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Under review as a conference paper at ICLR 2027

SkillAdm: Rubric-Guided, Skill-Specific Admission for Online Test-Time Skill Learning

Abstract

Online test-time skill learning (TTSL) enables frozen LLM agents to acquire reusable skills through interaction, continuously reusing and updating them over sequential task streams. Since a skill distilled from limited experience is not necessarily beneficial, skill admission—determining whether a candidate skill improves task execution before activating it for reuse—is critical for reliable online TTSL. Existing admission methods face two key challenges: coarse, oracle-free evaluation and validation limited to existing tasks. To address these, we propose SkillAdm, an online TTSL framework for continual agent self-improvement that acquires verified environment knowledge, constructs task-specific, progress-aware rubrics for oracle-free skill distillation, and performs two-stage utility assessment over both skill-specific validation tasks and relevant future verification tasks. Experiments across three benchmarks and three LLM backbones show that SkillAdm consistently outperforms the oracle-free baseline ASI and even surpasses oracle-assisted baselines using ground-truth outcomes.

Primary area:
applications to robotics, autonomy, planning
Keywords:
large language model agents, test-time skill learning, skill admission, rubric-guided evaluation, agent memory

Reviews

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1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_YQ6BOpenReview ↗
Rating
2
Confidence
2
Informativeness
1
Presentation
3
Soundness
3
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Paper summary

This paper proposes SkillAdm, an oracle-free framework for online test-time skill learning in frozen LLM agents. It uses verified environment knowledge and task-specific, progress-aware rubrics to guide skill distillation, followed by admission through validation on constructed skill-specific tasks and independent verification on relevant future tasks. The evaluation covers three benchmarks and three LLM backbones, with analyses of admission quality, rubric design, and cross-backbone skill transfer.

Critical strengths
  1. The paper highlights an important limitation of existing validation task pools. As discussed in Appendix A.2 and Introduction, source tasks, historical tasks, and fixed validation pools may provide limited coverage of the capability targeted by a candidate skill. Constructing executable, skill-specific validation tasks is a useful response to this limitation. This perspective is particularly relevant to continual learning, where historical tasks may also become unavailable.
  2. The empirical analysis examines both overall performance and the mechanisms underlying skill admission. The component ablations and rubric comparisons provide evidence for the benefits of verified environment knowledge, progress-aware evaluation, and the significance criterion. The appendix further illustrates the distillation and admission pipeline through a concrete case study, while the cross-backbone experiments support the transferability of the learned skills.
Critical weaknesses

The methodological novelty appears limited relative to the integration of established components. Hypothesis-driven exploration appears conceptually related to curiosity-driven exploration, while LLM-based scoring and contrastive distillation resemble established ideas in LLM evaluation and preference learning, including RLHF/RLAIF. Section 2.3 also explicitly builds on prior contrastive skill distillation. Although the distinction between constructed skill-specific validation and independent future-task verification is useful and empirically supported, I am not yet convinced that this decomposition constitutes a substantial methodological advance beyond combining and adapting existing ideas.

Questions for authors
  1. Rubric construction and prompting. Section 2.3 describes the rubric structure, and Appendix D/Table 5 provides an example. Could the authors provide the actual prompt or template used by the Judge to generate these rubrics, including the required inputs, constraints on criterion construction, and output schema? This would clarify how the illustrated rubric is produced reproducibly.
  2. Performance relative to oracle-assisted baselines. In the settings where SkillAdm outperforms GRASP and HDSO in Table 1, what accounts for the advantage despite their access to ground-truth outcomes? In particular, how should these gains be attributed to progress-aware evaluation versus differences in skill generation, validation tasks, and admission procedures?
  3. Outcome matching and robustness in knowledge validation. In Section 2.2, how is an observed transition determined to “exhibit” the expected outcome o^h\hat{o}_h or the contradictory outcome oh−o_h^{-}? Is this based on exact matching, semantic judgment, or another operational criterion? How are partially matching or ambiguous observations handled, and how robust is the supporting/refuting classification to observation noise or judgment errors?
5 comments
AuthorsOpenReview ↗

Response to Reviewer YQ6B (1/2)

We sincerely thank the reviewer for the careful evaluation and constructive feedback. We appreciate the recognition of our motivation and experimental analysis. We hope the following responses clarify our methodological contributions and implementation details.

W1: Limited methodological novelty beyond existing components.

Thank you for raising this concern. We acknowledge that some individual components of SkillAdm are related to established ideas in prior research. However, our contribution goes beyond combining existing techniques: we address two fundamental challenges in skill admission, namely, reliable utility assessment without oracle outcomes and skill validation beyond existing task pools. Our methodological contributions are as follows

First, task-specific, progress-aware rubrics. Unlike direct LLM correctness judgments, our task-specific rubrics evaluate both intermediate task progress and final goal completion, rather than relying solely on binary correctness judgments. They are constructed from task specifications, initial observations, and verified environment knowledge, providing fine-grained evaluation signals without official outcomes. As shown in Table 4 (Section 4.4), our rubric design substantially improves alignment with official benchmark outcomes, achieving gains of 9.67, 16.33, and 10.87 percentage points in pairwise accuracy over direct LLM judgment on ALFWorld, ScienceWorld, and BabyAI, respectively.

Second, skill-specific validation task construction. Unlike existing methods that rely on source tasks, historical tasks, or pre-allocated validation pools, SkillAdm constructs executable validation tasks tailored to each candidate skill using its description, supporting trajectory evidence, and verified environment knowledge. This enables direct assessment of skill utility in scenarios designed to exercise the skill’s intended capabilities, rather than limiting validation to existing tasks. The importance of this stage is supported by Table 3 (Section 4.2): removing Skill-Specific Utility Validation decreases performance by 5.48, 5.46, and 3.00 points on ALFWorld, ScienceWorld, and BabyAI, respectively. We have further clarified these methodological distinctions in Section 2 and added Table 1 to compare representative skill admission methods. Together, these designs address the challenges of oracle-free utility evaluation and skill validation beyond existing task pools, rather than simply combining established components.

Q1: Rubric construction and prompting details.

Thank you for this question. We have provided the complete rubric construction prompt and output schema in Appendix D.4. Beyond rubric construction, to further improve the reproducibility of SkillAdm, we also provide the prompts and corresponding output schemas for all five roles in Appendix D.

First, rubric construction. The Judge receives the task goal, initial observation, and verified environment knowledge. The Judge generates up to three ordered progress criteria and one goal criterion. To ensure that the progress criteria capture meaningful intermediate progress, each must be observable, directly relevant to the task goal, distinct from the others, and strictly weaker than complete task achievement. Accordingly, progress criteria must capture meaningful progress toward the task goal, rather than generic activities that may occur during task execution, such as navigation, searching, or inspection. In contrast, the goal criterion specifies the complete task objective, preserving all original requirements regarding the target objects, required actions, and final destination.

Second, output format. The Judge returns a structured list of criteria, each containing its role, name, description, and references to relevant environment knowledge. Importantly, the Judge does not receive the candidate skill during rubric construction, ensuring that the rubric is independent of the skill being evaluated.

AuthorsOpenReview ↗

Response to Reviewer YQ6B (2/2)

Q2: Performance improvements and attribution to individual components.

Thank you for raising this important question. We attribute SkillAdm's performance gains to two key contributions: task-specific, progress-aware rubrics and a two-stage skill admission mechanism.

First, regarding the underlying mechanism, access to ground-truth outcomes provides reliable task-level feedback, but does not necessarily ensure that the validation tasks adequately assess a candidate skill's intended capability. Existing oracle-assisted methods such as GRASP and HDSO rely on historical tasks or pre-allocated validation pools, which may not sufficiently exercise the capability targeted by each skill. In contrast, SkillAdm constructs skill-specific validation tasks to directly assess candidate utility and further verifies whether this utility transfers to relevant future tasks. Meanwhile, progress-aware rubrics capture intermediate task progress and final goal completion, providing fine-grained evaluation signals even without oracle access. These mechanisms help SkillAdm outperforming methods with access to ground-truth outcomes.

Second, regarding experimental evidence, we conduct controlled ablation experiments to examine the contributions of these components. Table 3 (Section 4.2) reports the relevant results.

VariantALFWorldScienceWorldBabyAI
Full78.4732.1622.00
w/o-Rubric74.09 ↓ 4.3830.18 ↓ 1.9820.50 ↓ 1.50
w/o-SkillVal.72.99 ↓ 5.4826.70 ↓ 5.4619.00 ↓ 3.00
w/o-FutVerif.67.88 ↓ 10.5927.36 ↓ 4.8020.50 ↓ 1.50
w/o-BothVerif.61.31 ↓ 17.1623.19 ↓ 8.9716.75 ↓ 5.25

Removing rubric-based evaluation consistently reduces task performance, while Table 4 (Section 4.4) further demonstrates that progress-aware rubrics achieve better alignment with official benchmark outcomes than Direct-Judge and Goal-Only evaluation. Moreover, removing either admission stage degrades performance, with the largest declines occurring when both stages are removed. These results support the contributions of progress-aware evaluation and two-stage skill admission to SkillAdm's effectiveness.

Q3: Outcome matching and robustness in environment knowledge validation.

Thank you for this question. We have provided the detailed evidence assessment procedure in Appendix A and the corresponding Explorer prompt and output schema in Appendix D.2.

First, outcome matching. For each record that directly tests a hypothesis, the Explorer checks whether the initial observation matches the hypothesis context, whether the expected outcome was absent before the action, and whether the environment successfully executed the proposed action. Only after these conditions are satisfied does the Explorer compare the resulting observation with the expected and contradictory outcomes specified by the hypothesis. Specifically, these assessments rely on LLM-based semantic judgments.

Second, ambiguous observations. Each evidence record is classified as supporting, refuting, or inconclusive. A record is supporting only when the observation explicitly demonstrates the expected outcome, and refuting only when it explicitly demonstrates the contradictory outcome under valid test conditions. Partially matching, ambiguous, or insufficient observations are classified as inconclusive rather than being treated as positive or negative evidence. The Explorer prompt requires the judgments to be grounded in observations before and after the action.

Thank you for the clarifications and additional evidence. I find the clarified methodological contribution acceptable and appreciate the general task-construction guidance in Appendix D.8. The component ablations and rubric-evaluation results sufficiently address my concerns about the utility of the proposed designs: both admission stages contribute to performance, and progress-aware rubrics improve alignment with benchmark outcomes, particularly intermediate progress in ScienceWorld.

My remaining questions concern implementation and reliability. Could the authors provide concrete task-construction and feasibility-checking procedures for ScienceWorld and BabyAI, including how generated objectives and initial states are instantiated and how goal reachability is checked? It would also be helpful to outline practical principles for adapting this procedure to a new environment, including the required environment capabilities and any environment-specific components. Finally, while the semantic matching rules and treatment of ambiguous evidence are now clearer, quantitative robustness evidence would strengthen the response—for example, supporting/refuting/inconclusive classification accuracy and repeated-judgment consistency under observation noise, paraphrasing, and incomplete or ambiguous observations.

Reviewer_1p3COpenReview ↗
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2
Confidence
1
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper proposes SkillAdm, an oracle-free framework for online test-time skill learning in frozen LLM agents. It combines verified environment knowledge, progress-aware rubric-guided skill distillation, and two-stage skill admission using synthesized skill-specific validation tasks and naturally occurring future tasks. Experiments across three benchmarks and three LLM backbones demonstrate improvements over existing oracle-free methods and competitive performance against oracle-assisted approaches.

Critical strengths
  • The paper addresses an important practical challenge in online skill learning, namely preventing unreliable skills from contaminating subsequent agent behavior.

  • The combination of progress-aware rubrics and skill-specific validation tasks provides a principled approach to assessing skill utility without ground-truth outcomes.

  • The experiments cover multiple benchmarks and model backbones, with ablation studies and cross-backbone transfer results supporting the effectiveness of the proposed components.

Critical weaknesses
  • Appendix B.1 introduces substantial additional environment exploration, multiple trajectory samples, and paired validation executions, yet only per-task interaction limits and Solver settings are stated to be controlled. Without reporting and matching total inference and environment interaction costs, the gains in Table 1 may partly reflect additional computation rather than better skill admission.
  • Section 2.4 and Figure 9 describe synthesized validation tasks using objectives and initial observations, but do not explain how these descriptions are instantiated as executable, reproducible states in the actual simulators.
  • Since skill-specific validation is a central contribution, the lack of a concrete task initialization and feasibility verification mechanism raises serious reproducibility concerns.
Questions for authors

see wekaness.

4 comments
AuthorsOpenReview ↗

Response to Reviewer 1p3C

We sincerely thank the reviewer for the careful evaluation and constructive feedback. We have added additional experiments and implementation details to address the concerns raised. We hope the following responses clarify our methodology and experimental findings.

W1: Computational cost and resource-matched evaluation.

Thank you for raising this concern. We have added computational cost analyses and additional control experiments in Appendix C.1–C.2 of the revised manuscript.

First, computational cost. We report the total LLM calls and token consumption of each method on ALFWorld using Qwen3.6-35B. Table 7 presents the results.

MethodCallsTokens (M)Task Performance (%)
No Skill--55.47
GRASP89,555478.69579.56 ↑ 24.09
HDSO64,822219.15273.36 ↑ 17.89
ASI45,828741.97065.69 ↑ 10.22
SkillAdm322,6371,204.52478.47 ↑ 23.00

Although SkillAdm consumes 1.62 times as many tokens as ASI, it achieves 2.25 times the held-out performance gain over No Skill. Table 8 further breaks down the computational costs across stages, showing that trajectory sampling and paired evaluations account for most of the overhead. These additional evaluations allow SkillAdm to assess candidate skill utility more carefully before skill admission.

Second, additional computation control. To examine whether SkillAdm's performance gains primarily result from increased computation, we introduce No Skill + Sampling, which increases the number of sampled trajectories without maintaining skill memory. Figure 6 (Appendix C.2) shows that performance plateaus at around 72% even with 24 sampled trajectories, remaining below SkillAdm's 78.47%. These results suggest that simply increasing the number of sampled trajectories is insufficient to match SkillAdm's performance, highlighting the contribution of its skill learning mechanism.

W2: Skill-specific validation-task construction.

Thank you for raising this concern. We have expanded the description of Skill-Specific Validation Task Construction in Section 3.4 and added a concrete example in Appendix C.6 (Figures 11–12) of the revised manuscript. For each candidate skill, the Proposer generates validation-task proposals based on the skill description, its supporting trajectory evidence, and verified environment knowledge. Each proposal specifies a task objective and an initial state. We then deterministically compile these proposals into the environment's native task definition. For example, Figure 11 presents an ALFWorld validation-task proposal involving heating a mug, while Figure 12 shows its corresponding PDDL problem.

W3: Feasibility and reproducibility of generated validation tasks.

Thank you for raising this concern. We would like to clarify that SkillAdm does incorporate explicit task initialization and feasibility verification mechanisms, although the original manuscript did not describe them in sufficient detail. We have therefore expanded Section 3.4 to make these mechanisms and the associated acceptance criteria explicit. Specifically, each validation-task proposal specifies a task objective and an initial state, together with references to the supporting source evidence and verified environment knowledge. We deterministically compile each proposal into the environment’s native task definition (e.g., a PDDL problem in ALFWorld), which instantiates the proposed initial state and encodes the objective as the goal condition. A task is accepted only if the candidate skill is applicable to the proposed scenario and can affect task execution, its actions and expected outcomes are grounded in the cited evidence, and the compiled task can be reproducibly initialized with a reachable goal. Tasks failing any of these checks are discarded. For each accepted task, we independently initialize the environment to the same specified initial state and evaluate the agent with and without the candidate skill. This controlled comparison ensures that the measured utility reflects the contribution of the candidate skill rather than differences in task initialization.

Thank you to the authors for their detailed response, which has addressed some of my concerns. Taking into account the other reviewers' comments and the authors' rebuttal, I have decided to maintain my original score.

AuthorsOpenReview ↗

Response to Reviewer 1p3C (1/2)

We thank the reviewer for their further assessment. We respect the reviewer's decision and would like to provide additional experimental evidence and implementation details that have been incorporated into the latest revision.

W1: Computational cost and resource-matched evaluation.

Reduced Computational Budget. To investigate whether SkillAdm's performance gains depend on a large computational budget, we evaluate SkillAdm under reduced budgets on ALFWorld using Qwen3.6-35B. Specifically, we vary the number of trajectories sampled per online task for skill distillation, setting K∈{1,3,5}K \in \{1, 3, 5\}. When K=1K = 1, a skill is directly distilled from the single sampled trajectory without cross-trajectory comparison. Table 10 reports the total LLM calls, token consumption, task performance, and number of active skills under different sampling budgets.

KKCallsTokens (M)Task performance (%)Active skills
5322,6371,204.52478.4721
3143,603803.90170.0713
192,176427.77965.694

As shown in Table 10, we observe two key findings.

  1. Reducing KK substantially decreases LLM calls and token consumption, but also lowers task performance, suggesting that sampling more trajectories facilitates the identification and distillation of high-quality skills. Notably, even with K=1K = 1, SkillAdm matches ASI's task performance while consuming only 57.66% of its tokens (a 42.34% reduction). This result shows that SkillAdm can distill and admit useful skills even under a limited sampling budget.

  2. As KK decreases, the number of active skills also drops substantially. This may be because a smaller KK provides fewer opportunities to identify high-quality candidate skills, while SkillAdm continues to filter out low-utility skills. Consequently, fewer skills are activated for reuse, which may partly explain the decline in task performance.

AuthorsOpenReview ↗

Response to Reviewer 1p3C (2/2)

W2: Skill-specific validation-task construction.

We have added detailed environment-specific procedures in Appendix B.

ALFWorld. ALFWorld represents household manipulation tasks as PDDL problems, which specify task objects, initial states, and goal conditions through the :objects, :init, and :goal blocks, respectively. Each proposal is compiled into a PDDL problem by declaring the typed objects referenced in the proposal in :objects, encoding its initial state in :init, and translating its objective into :goal. To check goal reachability, we use a PDDL planner to search for an action sequence that achieves the specified goal. If such a sequence is found and the conditions in Section 3.4 are satisfied, the proposed task is accepted for validation.

ScienceWorld. ScienceWorld represents scientific reasoning tasks in an interactive simulator that models rooms and their connections, objects and their properties, initial states, and goal conditions. We instantiate each proposal by constructing the specified rooms, placing the agent and objects at their initial locations, setting the object properties, and binding the goal conditions to the corresponding objects. To check goal reachability, the Proposer generates a candidate action sequence from the proposed initial state. We execute this sequence in the simulator and check whether the resulting state satisfies the goal conditions. If the goal is reached and the conditions in Section 3.4 are satisfied, the proposed task is accepted for validation.

BabyAI. BabyAI represents instruction-following tasks through grid-based environments and natural-language missions. We instantiate each proposal by constructing its room layout, setting the door states, placing the objects, and initializing the agent at the specified position and orientation. We translate the objective into a native BabyAI instruction. To check goal reachability, we use BabyAIBot, a built-in rule-based expert planner, to search for an action sequence that completes the instruction from the proposed initial state. If such a sequence is found and the conditions in Section 3.4 are satisfied, the proposed task is accepted for validation.

W3: Feasibility, reproducibility, and generalization to new environments.

Generalization to New Environments. Extending SkillAdm to a new environment requires three capabilities: (1) constructing executable tasks from proposed objectives and initial states, (2) reproducibly initializing tasks for paired executions, and (3) checking goal reachability through available environment actions. Two components require environment-specific implementation. The task constructor translates the proposed objective and initial state into the environment's native task definition. The reachability checker can use a planner, an expert agent, or simulator-based execution of a candidate action sequence. Proposals are rejected if they cannot be reliably instantiated or if goal reachability cannot be verified. The remaining SkillAdm components, including skill-specific proposal generation, rubric-guided evaluation, and two-stage skill admission, follow the same general procedure across environments.

Reviewer_CWhmOpenReview ↗
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2
Confidence
3
Informativeness
2
Presentation
3
Soundness
3
Read review
Paper summary

The paper studies skill admission in online test-time skill learning (TTSL): before a skill distilled from interaction trajectories enters the retrievable skill memory, the system must decide whether it actually improves execution. The authors identify two limitations of existing admission methods — (L1) coarse oracle-free evaluation, and (L2) validation confined to pre-existing tasks — and propose SkillAdm: hypothesis-driven exploration yields verified state–action–outcome knowledge; that knowledge and the task specification are used to build task-specific, progress-aware rubrics that score trajectories without ground truth; Action and Avoidance skills are distilled contrastively from high-quality vs. near-miss trajectories; and a skill is admitted only if paired, rubric-scored evaluation passes a mean-margin and significance test on both constructed skill-specific tasks and relevant future tasks from the stream. Experiments on ALFWorld, ScienceWorld and BabyAI with three frozen backbones (Qwen3.6-35B, Gemma-4-26B, GPT-OSS-120B) show gains over ASI and over oracle-assisted baselines in some settings.

Critical strengths
  1. Clear problem decomposition. Separating admission from distillation, and splitting the difficulty into L1/L2 with one module per challenge, gives the reader a compact mental model. Figures 1–2 make the contrast with prior work immediate.
  2. Good presentation. The figures are informative, the case study (App. D) makes the mechanism concrete, and the paper is easy to follow despite a dense §2–§3.
  3. Stronger backbones than is typical. Three models at 26B–120B rather than sub-10B, and the cross-backbone transfer study (RQ5) addresses a question practitioners actually have — whether memory built on a cheap model can serve a stronger one.
  4. Systematic ablation on the admission side, and the finding that a mean utility margin alone is insufficient (w/o-SigCrit, −12.05 on ALFWorld) is a genuinely useful observation.
Critical weaknesses

W1 — Headline claims are not supported at the reported margins. No seeds, standard deviations, or confidence intervals appear in Table 1. The abstract-level claim that SkillAdm "surpasses oracle-assisted baselines" rests on 0.25–0.5 point differences (BabyAI/Qwen: 22.00 vs 21.50; BabyAI/Gemma: 21.75 vs 21.50) and 1–1.4 points on ScienceWorld. The paper demands p ≤ 0.05 p≤0.05 of every skill it admits but reports no significance for its own conclusions.

W2 — The controls that would isolate the cause are missing. There is no admit-all variant (both gates removed), no information-parity baseline (same environment knowledge B B or documentation in context, without the admission machinery), and no test-time-compute parity condition (No Skill given an equal rollout or sampling budget). Because skill gains are concentrated where the base model is weak, the compute-parity comparison is the one that decides whether the method contributes knowledge or merely reallocates inference.

W3 — Three benchmarks are effectively one environment class. All are text-observation, discrete-action, turn-based, resettable, and programmatically scored. There is also a circularity: admission quality (AR/UAR/USR/HAR) is labeled using official benchmark outcomes, i.e. an oracle is used to evaluate an oracle-free method, and the rubric itself is validated (RQ4) only where ground truth exists — precisely the condition the method claims not to require.

W4 — Cost is asserted, not measured, and the design assumes free resets. No token, call-count, or wall-clock table is given, yet one admission decision costs 12 proposals plus N fut

80 N fut =80 future tasks × with/without × ≤50 turns ≈ 160 rollouts per skill. Two consequences go unaddressed: paired evaluation requires resetting to the same initial observation, which most real environments do not allow; and the rule "discard the skill if fewer than 80 relevant future tasks are found" silently empties the memory in a heterogeneous stream.

W5 — The ablation is asymmetric. Six variants cover the admission side, but §2.3 has three unablated design decisions: contrastive vs. positive-only distillation, near-miss filtering ( η η), and the Action/Avoidance split. The ablation is also Qwen-only.

W6 — Single signal source with a confound. Judge, Solver, Distiller and Proposer share one backbone. Rubric scores are the only signal in the pipeline, and self-preference bias is not removed by anonymizing trajectories as X/Y. No inter-rater agreement or judge calibration is reported.

W7 — No real-scenario design. The rubric is generated from the task specification, so the method depends on clean, well-formed goals; skills are non-executable prose; dynamics are assumed resettable; there is no retirement or drift handling and no defined criterion for merging conflicting skills. For the applications the framing implies (e.g. agentic coding), none of these holds, and nothing in the design targets them. The gap is therefore not only "not yet evaluated there" but "designed not to go there."

W8 — Structure. Related work in the appendix is a real cost in a fast-moving subfield: it removes the positioning that the contribution needs. §2.2's formalization, the near-duplicate threshold derivations (Eqs. 5–8), and the metric definitions in §3.3 could move to the appendix, freeing ~2 pages for a positioning table (method × validation-task source × evaluation signal × oracle requirement) that would do more for the paper than the current prose.

Questions for authors
  • (W1) Please report mean ± std over ≥3 seeds for Table 1. Are the BabyAI margins statistically distinguishable from GRASP/HDSO?
  • (W2) What is the admit-all result? And does SkillAdm's advantage survive when No Skill receives an equal rollout/sampling budget?
  • (W6) How do results change with a judge from a different model family? What is the judge's agreement rate with benchmark outcomes?
  • (W3) Without official outcomes, how would UAR/USR/HAR be estimated in deployment — i.e. what validates the validator?
  • (W4) What fraction of candidate skills satisfies N=80 on each benchmark? Could you plot admission rate, memory size and marginal gain against task index to show where the memory saturates?
  • (W4) What is the per-skill cost in LLM calls, tokens and environment steps, and the resulting cost per success point?
  • (W5) What is the effect of positive-only distillation and of removing Avoidance skills?
9 comments
AuthorsOpenReview ↗

Response to Reviewer CWhm (1/6)

We sincerely thank the reviewer for the careful evaluation and constructive feedback. We have conducted additional experiments and revised the manuscript to address the concerns raised. We hope the following responses clarify our contributions and address the reviewer's questions.

W1&Q1: Small performance margins and lack of multi-seed evaluations.

Regarding the small performance margins, we first clarify the role of each baseline in our evaluation. ASI is the most directly comparable baseline to SkillAdm, as both operate without ground-truth outcome supervision. In contrast, GRASP and HDSO rely on ground-truth outcomes for skill utility assessment. We include them as oracle-assisted references to contextualize the performance of SkillAdm against methods with access to additional supervision, rather than as directly comparable baselines. As shown in Table 2, SkillAdm consistently outperforms ASI, the directly comparable oracle-free baseline, across all nine benchmark–backbone combinations, with improvements ranging from 2.75 to 17.51 points. More importantly, despite not accessing ground-truth outcomes, SkillAdm also matches or surpasses the oracle-assisted baselines in several settings, including gains of 5.47 points over the strongest oracle-assisted baseline on ALFWorld with GPT-OSS and 1.70 points on ScienceWorld with GPT-OSS. These results demonstrate the effectiveness of SkillAdm as an oracle-free skill admission method, consistently outperforming the directly comparable oracle-free baseline while achieving performance comparable to or better than oracle-assisted approaches in several settings.

Regarding the request for multiple seeds, we acknowledge that multi-seed evaluation would provide a more comprehensive assessment of performance variability. We note that recent works in related agent memory research, including ReasoningBank (ICLR 2026) [1], SimpleMem (ICML 2026) [2], and MemSkill (NeurIPS 2026) [3], also report benchmark results without multi-seed standard deviations. Nevertheless, we agree that this remains a limitation of our evaluation. Accordingly, without multi-seed results, we refrain from claiming statistical significance for the small performance margins over GRASP/HDSO on BabyAI. Importantly, SkillAdm achieves consistent and substantial improvements over the directly comparable oracle-free baseline ASI across all nine benchmark–backbone combinations, with gains of 2.75–17.51 points. This consistent advantage, together with its competitive performance against oracle-assisted methods, supports the effectiveness of SkillAdm.

Reference

[1] Ouyang, Siru, et al. "ReasoningBank: Scaling Agent Self-Evolving with Reasoning Memory." ICLR 2026.

[2] Liu, Jiaqi, et al. "SimpleMem: Efficient Lifelong Memory for LLM Agents." ICML 2026.

[3] Zhang, Haozhen, et al. "MemSkill: Learning and Evolving Memory Skills for Self-Evolving Agents." NeurIPS 2026.

AuthorsOpenReview ↗

Response to Reviewer CWhm (2/6)

W2&Q2: Missing control experiments for skill admission, environment knowledge, and additional computation.

Thank you for these suggestions. We have conducted additional control experiments to better isolate the sources of SkillAdm's performance gains.

First, admit-all control. We evaluate w/o-BothVerif., which removes both admission stages and admits all generated skills. The relevant results from Table 3 are shown below.

VariantALFWorldScienceWorldBabyAI
Full78.4732.1622.00
w/o-BothVerif.61.31 ↓ 17.1623.19 ↓ 8.9716.75 ↓ 5.25

As further shown in Figure 4 in the paper, this variant yields nearly equal UAR and HAR, indicating that it admits nearly as many harmful skills as useful ones. Combined with the substantial declines in task performance, this suggests that the negative impact of harmful skills may outweigh the benefits of useful skills, further highlighting the importance of filtering harmful skills before reuse. We have added these results in Table 3 (Section 4.2).

Second, environment knowledge control. On ALFWorld with Qwen3.6-35B, we construct No Skill+B by directly providing verified environment knowledge to the Solver as execution context, without maintaining a skill memory. Table 9 (Appendix C.2) reports the results.

MethodSkill MemoryTask Performance (%)
No Skill✗55.47
No Skill+B✗56.93
w/o-EnvKnow.✓72.63
SkillAdm✓78.47

Directly providing environment knowledge yields only a marginal improvement over No Skill, whereas w/o-EnvKnow. still substantially outperforms the strongest oracle-free baseline, ASI. These results indicate that SkillAdm's gains cannot be explained by additional environment knowledge alone.

Third, additional sampling control. We introduce No Skill + Sampling, which samples multiple trajectories and uses an LLM-based Judge to select the best candidate trajectory without skill memory. As shown in Figure 6 (Appendix C.2), performance improves initially but plateaus at around 72% as the number of sampled trajectories increases, remaining below SkillAdm's 78.47% even with 24 trajectories. These results suggest that additional inference-time sampling alone is insufficient to match the benefits of learned skill memory under the evaluated settings. We have added these experiments and analyses to Section 4.2 and Appendix C.2 of the revised manuscript, with the additions highlighted in blue.

W3&Q4: Benchmark selection and oracle-free evaluation.

Thank you for raising these concerns.

First, benchmark selection. Following prior work such as SkillGen (Ding et al., AAAI 2026) [1] and AgentBoard (Ma et al., NeurIPS 2024) [2], we evaluate SkillAdm on ALFWorld, ScienceWorld, and BabyAI, covering household manipulation, scientific reasoning, and grounded instruction following, respectively. These environments provide observable state–action–outcome transitions and multi-step interactions, enabling controlled evaluation of skill learning and admission. We acknowledge that extending SkillAdm beyond simulated interactive environments remains an important direction for future work.

Second, circularity. We clarify that UAR, USR, and HAR are evaluation metrics, not signals used by SkillAdm for online skill admission. During deployment, SkillAdm does not need to estimate these metrics or access official outcomes. Instead, all admission decisions rely exclusively on Skill-Specific Utility Validation and Decoupled Online Utility Verification (Sections 3.4–3.5). Official benchmark outcomes are used only for post-hoc evaluation of admission quality. The detailed evaluation protocol for computing UAR, USR, and HAR using official benchmark outcomes is provided in Appendix B.

Finally, evaluation without oracle access. While UAR, USR, and HAR are only needed for post-hoc evaluation and not for SkillAdm’s deployment, if their estimation is desired in real-world settings, utility labels could be approximated through majority voting among multiple LLM evaluators or stronger external models, such as Claude Opus 5.5.

Reference

[1] Ding, Ruomeng, et al. "SkillGen: Learning Domain Skills for In-Context Sequential Decision Making." AAAI 2026.

[2] Ma, Chang, et al. "AgentBoard: An Analytical Evaluation Board of Multi-turn LLM Agents." NeurIPS 2024.

AuthorsOpenReview ↗

Response to Reviewer CWhm (3/6)

W4: Computational cost, environment resets, and skill memory management.

Thank you for raising these concerns. We have added computational cost analyses and skill admission statistics to the revised manuscript.

First, computational cost. We evaluate SkillAdm's computational cost on ALFWorld using Qwen3.6-35B. Table 7 (Appendix C.1) reports the total LLM calls and token consumption of each method.

MethodCallsTokens (M)Task Performance (%)
No Skill--55.47
GRASP89,555478.69579.56 ↑ 24.09
HDSO64,822219.15273.36 ↑ 17.89
ASI45,828741.97065.69 ↑ 10.22
SkillAdm322,6371,204.52478.47 ↑ 23.00

Although SkillAdm consumes 1.62 times as many tokens as ASI, it achieves 2.25 times the task performance gain over No Skill. Table 8 further provides a detailed breakdown of computational costs across different stages, showing that trajectory sampling and paired skill evaluations account for most of the overhead.

Second, environment resets. In our benchmarks, paired evaluations are performed by independently initializing the same task for executions with and without each candidate skill. For real-world applications, such as software engineering, web automation, and enterprise workflow management, which are among the widely adopted application domains for agents, paired evaluations could be conducted in isolated sandbox environments or simulated replicas, allowing controlled comparisons without affecting production systems. However, in real-world applications such as real-time customer service interactions where reproducible initialization is unavailable, exact paired evaluations may not be feasible. We have acknowledged this limitation in the revised manuscript and left it as a potential direction for future work.

Finally, emptying skill memory. We clarify that discarding a candidate skill does not mean deleting it, but rather excluding it from the active skill memory used for retrieval. Previously admitted skills remain available for subsequent tasks. Figure 7 (Appendix C.4) further shows that active skill memory continues to grow throughout online learning, demonstrating that the verification requirement does not empty skill memory.

W5&Q7: Skill distillation ablations, near-miss filtering, and backbone coverage.

Thank you for these suggestions. We have added two additional ablation variants to Table 3 (Section 4.2) of the revised manuscript.

First, skill distillation ablations. We evaluate w/o-AvoSkill., which removes Avoidance skill generation while retaining contrastive Action skill distillation, and w/o-NearMiss., which removes near-miss trajectories. The relevant results from Table 3 are shown below.

VariantALFWorldScienceWorldBabyAI
Full78.4732.1622.00
w/o-AvoSkill.77.37 ↓ 1.1031.01 ↓ 1.1521.75 ↓ 0.25
w/o-NearMiss.73.36 ↓ 5.1128.15 ↓ 4.0121.00 ↓ 1.00

Removing Avoidance skills causes relatively minor performance decreases, indicating their modest contribution. According to our statistics, Avoidance skills account for only approximately 4% of all distilled skills. This small proportion may partly explain their limited contribution to overall task performance. In contrast, removing near-miss trajectories leads to larger decreases across all three benchmarks. This comparison further highlights the contribution of near-miss trajectories to skill distillation.

Second, near-miss filtering. Figure 8 (Appendix C.5) already provides a sensitivity analysis of the action-pattern similarity threshold η\eta. The results show that overly strict filtering reduces performance by excluding informative near-miss trajectories.

Finally, backbone coverage. Our main experiments evaluate SkillAdm across three benchmarks and three distinct LLM backbones, while the ablation studies use Qwen3.6-35B across all three benchmarks to isolate component contributions under consistent settings. Similar experimental designs are adopted in ReasoningBank (ICLR 2026) [1] and SimpleMem (ICML 2026) [2], both of which conduct ablation studies using a single representative backbone.

Reference

[1] Ouyang, Siru, et al. "ReasoningBank: Scaling Agent Self-Evolving with Reasoning Memory." ICLR 2026.

[2] Liu, Jiaqi, et al. "SimpleMem: Efficient Lifelong Memory for LLM Agents." ICML 2026.

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