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Under review as a conference paper at ICLR 2027

SkillScaffold: Scaffolding Agentic Reinforcement Learning with Policy-Adaptive Skill Credit Assignment and Selective Injection

Abstract

Agentic reinforcement learning (RL) enables large language models (LLMs) to learn from multi-turn interactions with verifiable outcomes. Textual skills can improve exploration by distilling prior interactions into reusable guidance. However, existing skill-based RL approaches often either assume skill injection is beneficial or rely on indirect feedback or rollout-intensive evaluation to assess its utility. Our pilot studies show that rollout-based utility estimation for skill credit assignment is costly and unstable under limited sampling, while skill benefits vary across candidates and depend on the current policy's competence on each query. To address these challenges, we introduce SkillScaffold, a policy-adaptive training scaffold that combines low-cost skill-utility estimation with selective skill injection. By reusing outcome-verified training trajectories, SkillScaffold generates candidate skills and estimates their utility through outcome-aware likelihood comparisons, without candidate-specific environment rollouts. The resulting utility guides whether and which skill to inject, retaining skill-free execution when no candidate is estimated to help. Joint training enables the Generator to produce skills tailored to the evolving Executor. Scaffolded RL encourages skill internalization for skill-free inference. Experiments on ALFWorld, WebShop, ScienceWorld, and -Bench demonstrate gains over strong agentic-RL and skill-based RL baselines across both short- and long-horizon tasks. Ablations and further analyses support the importance of utility-based selection and abstention.

Primary area:
foundation or frontier models, including LLMs
Keywords:
agentic reinforcement learning, large language model agents, textual skills, skill credit assignment

Reviews

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1234this paper, Top 49%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.33 over 3 reviews, above 51% of the others.
Reviewer_v4omOpenReview ↗
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2
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Paper summary

The paper introduces SkillScafold, a new method in Agentic RL which aims to improve skill generation and skill-free inference, by providing a novel training pipeline.

The authors highlight significant motivating observations, such as instability and high cost of rollout utility estimation, query and policy dependence of the rollout skill utility. Based on them, they provide a better way to estimate utility with group-based approach, based on probabilities of preferable trajectories rather than the rollout based utility. By jointly training a single model on both skill generation and skill-conditioned inference, and using proposed utility estimation method to select skill candidates, they achieve promising results on various benchmarks such as WebShop, ALFWorld, ScienceWorld and r^2-bench. In particular, they measure the internalization of skills by the model by providing skill-free benchmarks, which shows the positive effect of joint train.

Critical strengths
  1. The paper practically addresses when and which self-generated skill to inject in agentic RL. Section 3 empirically proves that skills can hurt performance depending on the current policy's strength. This idea matters because it is simple, cheap, and easily applicable to other hint-guided RL exploration methods.
  2. The method is thoroughly evaluated on four benchmarks, including the long-horizon r^2 benchmark, outperforming standard RL and deep variety of baselines. Significant work has been done in theoretical analysis, which makes deeper understanding on components of the method. This extensive evaluation makes the reported gains highly plausible and clearly isolates where the improvements come from.
  3. The paper is well-written, the motivating experiments section in general makes sense, despite the existence of weaknesses. Overall, the text makes deeper understanding of the problem even for people whose research is not much related to the field
Critical weaknesses
  1. The "motivating questions" experiments are model and dataset-specific. The concern is that specified Qwen3-8B, which was used across all experiments, may bring a model-specific bias in motivating questions formulation, because skill-guided and skill-free inference performance may vary across models. Alongside, the "non-saturated pilot subset" is of an undetermined nature: there is no evidence as to how it was formed. In the end, certain evaluations, such as disagreement dependence on K, may vary across different subsets, which make the pilot study biased.
  2. There is no ablations on effectiveness of group-based utility estimation in comparison with rollout based approach.
  3. The methodology of scouts-to-skills pipeline raises questions. There is no evidence on choosing 4 scout trajectories instead of another number and why are we passing only positive candidate instead of all (or one positive-one negative) candidates.
  4. Minor issues: N is not large enough for some benchmark on figure 4, WebShop is considered to be a relatively small benchmark in figure 4, which makes unreliable eval. In general, multiseed is conducted for comparison in WebShop and ALFWorld, because of small validation groups
  5. The GRPO and "no executor injection" setups (Table 1 and Table 3) differ only in existence of auxiliary loss; surprisingly, this yields a substantial performance boost (90.3 vs 85.6 ALFWorld, 41.5 vs 38.2 WebShop), which raises questions about how much of an improvement the skill injection mechanism contributes. In particular, that may be caused by divergence of configs the models were trained with.
Questions for authors
  1. Are the paper findings transferrable on different models? Can authors rerun some benchmarks (table 1, motivating expreriments) with different models, like qwen3-4b?
  2. Why do authors choose K=4 to execute skillscafold? How do performance and inference ablates on different K? Can authors provide
  3. It's not clear whether we exclude all-negative scenarios from r^2 benchmark or not. In general, the appendix say that we exclude all-success, all-failure tasks from r^2, but experiments like figure 12 considered to have them in dataset.
  4. Are the evaluation pipelines differs in Table 1 and Table 3? If so, are the configs of GRPO and "no executor injection" differs, and how much improvement the skill injection mechanism gives?
4 comments
AuthorsOpenReview ↗

Reply to Reviewer v4om(1/4)

Thank you for your careful review and constructive suggestions!

Summary. Your main concerns cover cross-model generalization, utility estimation, Scout-budget choices, evaluation reliability, and experimental protocols. We provide additional cross-model experiments, direct utility-estimation comparisons, Scout-budget ablations, and three-seed evaluations, alongside clarifications of pilot sampling, τ²-Bench filtering, and the controlled comparison of skill injection.


(1) W1 & Q1: Cross-Model Generalization and Pilot-Study Protocol

W1: The "motivating questions" experiments are model and dataset-specific. The concern is that specified Qwen3-8B, which was used across all experiments, may bring a model-specific bias in motivating questions formulation, because skill-guided and skill-free inference performance may vary across models. Alongside, the "non-saturated pilot subset" is of an undetermined nature: there is no evidence as to how it was formed. In the end, certain evaluations, such as disagreement dependence on K, may vary across different subsets, which make the pilot study biased.

Q1: Are the paper findings transferrable on different models? Can authors rerun some benchmarks (table 1, motivating expreriments) with different models, like qwen3-4b?

Response: Thanks for the question and suggestion.

1. Cross-model evaluation. To test transferability, we repeat the Table 1 comparisons using Qwen2.5-7B-Instruct, including GRPO, SkillRL, and the strongest skill-based RL baseline on each benchmark.

MethodALFWorld AVGWebShop AVG
ReAct45.1014.00
GRPO74.0035.60
SkillRL†78.9038.00
SKILL1†87.03—
Evolving-RL†—43.60
SkillScaffold*91.9846.60

(* denotes skill-free evaluation; † denotes evaluation with skills.)

SkillScaffold exceeds the strongest competing results by 4.95/3.00 percentage points on ALFWorld/WebShop, supporting its effectiveness beyond Qwen3-8B. Full category-level results are reported in Appendix B.2 of the revised manuscript.

2. Cross-model pilot validation. We have added two pilot experiments with Qwen2.5-7B-Instruct: rollout-based utility-estimation stability and within-query candidate-effect evaluation. At K=8K=8, independent rollout-based utility estimates disagree in sign for 29.9% of candidate–query pairs whose two estimates are both nonzero (72/241). Moreover, 40 of 100 queries contain candidates with both positive and negative measured downstream effects. These results support the motivating observations beyond Qwen3-8B. The additional results are reported in Appendix B.2 of the revised manuscript.

3. Pilot-subset construction. We clarify that the original non-saturated subset was randomly sampled from WebShop training queries whose skill-free success rate under the base Qwen3-8B model satisfies 20%≤SR≤80%20\% \leq \mathrm{SR} \leq 80\%, estimated using K=8K=8 rollouts per query. This criterion uses skill-free performance rather than candidate skill effects. We have added this sampling protocol to Appendix A.5 of the revised manuscript.

AuthorsOpenReview ↗

Reply to Reviewer v4om(2/4)

(2) W2: Comparison with Rollout-Based Utility Estimation

W2: There is no ablations on effectiveness of group-based utility estimation in comparison with rollout based approach.

Response: Thanks for the suggestion. We address this through a method-level comparison and an additional utility-estimation experiment.

1. Method-level comparison. Table 1 includes Evolving-RL, which evaluates skills through downstream environment rollouts. With Qwen3-8B, the results are:

MethodALFWorldWebShop
Evolving-RL†74.841.8
Evolving-RL*77.027.7
SkillScaffold*94.845.1
(* denotes skill-free evaluation; † denotes evaluation with skills.)

These method-level results show that SkillScaffold achieves higher success rates than the rollout-based baseline on both benchmarks without requiring candidate-specific environment evaluation.

2. Direct utility-estimation comparison. We extend the evaluation in Section 5.4, Figure 5(a), with rollout-based utility estimation. For each candidate skill, we sample KK trajectories on the corresponding task and use its empirical pass rate as the utility estimate. The highest-scoring candidate is selected and evaluated using separate downstream rollouts. With four candidates per query, this requires 4K4K additional candidate-evaluation rollouts.

Utility estimationExtra candidate-evaluation rollouts/queryDownstream success rate (%)
Likelihood utility + gated top-1067.6
Rollout utility, K=1K=1460.5
Rollout utility, K=2K=2860.0
Rollout utility, K=4K=41668.4
Rollout utility, K=8K=83267.8

Our likelihood-based utility exceeds rollout-based selection by 7.1/7.6 percentage points at K=1/2K=1/2. At K=4/8K=4/8, rollout-based selection achieves slightly higher success rates by 0.8/0.2 points, but requires 16/32 additional environment rollouts per query. Our method therefore provides competitive downstream performance without candidate-specific environment evaluation. We have added this direct utility-estimation comparison to Appendix B.7 of the revised manuscript.


(3) W3 & Q2: Scout Budget Hyperparameter Experiments

W3: The methodology of scouts-to-skills pipeline raises questions. There is no evidence on choosing 4 scout trajectories instead of another number and why are we passing only positive candidate instead of all (or one positive-one negative) candidates.

Q2: Why do authors choose K=4 to execute skillscafold? How do performance and inference ablates on different K? Can authors provide

Response: Thanks for the question and suggestion. We have added a Scout-budget ablation on WebShop. To keep the total number of Executor training rollouts per query fixed at eight, we vary the allocation between NN Scouts and LL Post-Scouts while fixing the candidate count at M=4M=4.

NN ScoutsLL Post-ScoutsWebShop success rate (%)
2639.33
4445.10
6237.82

With N=2N=2, fewer Scout trajectories may limit the availability of reliable evidence for skill generation and utility estimation. With N=6N=6, only two Post-Scout rollouts remain, reducing the proportion of potentially skill-guided trajectories in the Executor training group. The 4/4 allocation balances these two needs and performs best among the settings. We have added this Scout-budget ablation to Appendix B.6 of the revised manuscript.

AuthorsOpenReview ↗

Reply to Reviewer v4om(3/4)

(4) W4: Evaluation Reliability

W4: Minor issues: N is not large enough for some benchmark on figure 4, WebShop is considered to be a relatively small benchmark in figure 4, which makes unreliable eval. In general, multiseed is conducted for comparison in WebShop and ALFWorld, because of small validation groups

Response: Thanks for highlighting the importance of evaluation reliability. We would like to gently clarify that Figure 4 presents the architectural overview of SkillScaffold. To directly address the evaluation reliability on ALFWorld and WebShop, we report additional multi-seed comparisons below.

Tables 1–3 originally report single training runs, with Pass@1 estimated by averaging over k=8k=8 rollouts per task. To assess training-run variability, we reran SkillScaffold and the strongest skill-based RL baselines—SKILL1 on ALFWorld and Evolving-RL on WebShop—across three independent random seeds. The mean ± standard deviation results are:

BenchmarkMethodSuccess rate (%)
ALFWorldSkillScaffold*93.94 ± 0.74
ALFWorldSKILL1†90.30 ± 1.37
WebShopSkillScaffold*45.04 ± 1.30
WebShopEvolving-RL†40.60 ± 1.17

(* denotes skill-free evaluation; † denotes evaluation with skills.)

SkillScaffold exceeds the strongest baselines by 3.64/4.44 percentage points on ALFWorld/WebShop in mean performance. These repeated-run results strengthen the evidence for the consistency of the reported gains.


(5) Q3: Clarification of τ2\tau^2-Bench Filtering and Online Scout Outcomes

Q3: It's not clear whether we exclude all-negative scenarios from r^2 benchmark or not. In general, the appendix say that we exclude all-success, all-failure tasks from r^2, but experiments like figure 12 considered to have them in dataset.

Response: Thanks for the question. We would first clarify that the benchmark is τ2\tau^2-Bench.

We evaluate the post-SFT model on all training queries using eight rollouts per query, then exclude queries with 0/8 or 8/8 successes to retain queries with mixed observed outcomes for group-relative learning.

This initial filtering does not guarantee mixed outcomes in subsequent Scout groups. During training, we sample four fresh Scout trajectories per query at a nonzero temperature. Queries with an initial success rate of 1/8 or 2/8 can therefore yield all-wrong Scout groups, while those with 6/8 or 7/8 can yield all-correct groups. Thus, the all-wrong and all-correct groups in Figure 12 are consistent with our filtering protocol.

AuthorsOpenReview ↗

Reply to Reviewer v4om(4/4)

(6) W5 & Q4: Contribution of Skill Injection and Configuration Consistency

W5: The GRPO and "no executor injection" setups (Table 1 and Table 3) differ only in existence of auxiliary loss; surprisingly, this yields a substantial performance boost (90.3 vs 85.6 ALFWorld, 41.5 vs 38.2 WebShop), which raises questions about how much of an improvement the skill injection mechanism contributes. In particular, that may be caused by divergence of configs the models were trained with.

Q4: Are the evaluation pipelines differs in Table 1 and Table 3? If so, are the configs of GRPO and "no executor injection" differs, and how much improvement the skill injection mechanism gives?

Response: Thanks for raising this question. We clarify the configurations and distinguish the contributions of Generator learning and Executor skill injection below.

1. Evaluation pipeline and training configurations. Tables 1 and 3 use the same evaluation pipeline, test splits, decoding settings, and Pass@1 estimation with eight rollouts per task.

For training, GRPO uses a clipping parameter of 0.20 with a small KL penalty. SkillScaffold uses lower/upper clipping parameters of 0.20/0.28 and no KL penalty. These settings were chosen to accommodate joint Generator–Executor optimization with shared model parameters. Importantly, Full SkillScaffold and No Executor injection use identical training configurations and Executor rollout budgets.

2. Contribution of Generator learning. The "No Executor injection" variant is not merely standard GRPO with an auxiliary loss. Instead, it maintains the complete SkillScaffold training architecture: the policy is still actively trained to diagnose Scout trajectories, synthesize high-utility skills, and optimize skill-generation tokens via RL loss.

Through this active training loop, the model continuously encounters, generates, and refines skills. Because the Generator and Executor share underlying parameters, training the model to master skill synthesis directly instills robust task-abstraction and reasoning capabilities into the shared backbone. This explains why the variant outperforms standard GRPO even when prompt-level skill injection is withheld during Executor execution.

3. Controlled comparison of skill injection. Comparing Full SkillScaffold with No Executor injection retains Generator learning and strictly controls the training configuration:

Training setupALFWorld AVGWebShop AVG
No Executor injection90.341.5
Full SkillScaffold94.845.1
Additional gain+4.5 pp+3.6 pp

These results demonstrate an additional benefit from training-time Executor skill injection, beyond retaining Generator learning. Both variants are evaluated without skills.

For clarity, the quoted WebShop GRPO score of 38.2 is its ID score; its overall AVG is 36.5.


Thank you again for your constructive feedback, which helped us strengthen the evidence for cross-model generalization and evaluation reliability, add direct utility-estimation comparisons and hyperparameter experiments on Scout allocation.

Reviewer_Xz25OpenReview ↗
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Informativeness
2
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Paper summary

This paper introduces SkillScaffold, a training framework that uses textual skills to help LLM agents learn from interaction. The main idea is to estimate whether a skill will help by rescoring existing trajectories, rather than running additional environment evaluations for every candidate. The estimated utility determines which skill to inject and when to skip injection altogether. A shared model learns both skill generation and task execution, and the skill pathway is removed at inference. Experiments on ALFWorld, WebShop, ScienceWorld, and τ²-Bench show improvements over the reported RL and skill-based baselines.

Critical strengths

I like the decision to treat skill use as something the agent should be selective about. Generating plausible guidance does not necessarily mean that following it will help. Reusing existing trajectories to make this decision is a practical idea, and the ablations provide meaningful support: both random selection and removing abstention noticeably hurt performance.

The gains remain when skills are removed at inference, which makes the method useful beyond a more elaborate prompting setup. The reported improvements are consistent across several environments, including WebShop and long-horizon tool use. For example, WebShop improves from the strongest competing result of 41.8 to 45.1, while τ²-Bench improves from 60.0 for GRPO to 63.4 on average.

Critical weaknesses

The utility score needs stronger validation, especially when all Scouts fail. Making observed failures less likely could simply lead to different failures. Figure 5 is encouraging, but the gate’s reliability across benchmarks and training stages remains unclear.

The overall training-cost advantage is unclear. Candidate generation and trajectory rescoring add computation, but the paper does not report actual training time or comparisons under the same compute budget.

The mechanism analyses need better controls. In Figure 6, fresh samples could recover from all-wrong Scouts even without skills. Similarly, the later gains in Table 4 could partly reflect ordinary RL progress rather than skill internalization.

Questions for authors

How often does a positive utility score select a skill that actually reduces downstream success? A breakdown by Scout outcome group and training stage would help assess whether the zero threshold is reliable.

Were the RL baselines matched to SkillScaffold in environment interactions? What is the measured training overhead from candidate generation and trajectory scoring, and how do the methods compare at the same total compute budget?

For Figure 6, how much recovery occurs with four fresh skill-free rollouts on the same all-wrong queries and frozen policy? For Table 4, how does recovery on the same fixed cohorts compare with the no-Executor-injection variant?

4 comments
AuthorsOpenReview ↗

Reply to Reviewer Xz25(1/4)

Thank you for your careful review and constructive suggestions!

Summary. Your main concerns are utility reliability, total training costs and budget matching, and the controls for exploration and skill internalization. Below, we provide stratified downstream validation, measured training costs, and controlled comparisons that separate skill guidance from fresh sampling and continued training.


(1) W1 & Q1: Reliability of Positive-Utility Selection

W1: The utility score needs stronger validation, especially when all Scouts fail. Making observed failures less likely could simply lead to different failures. Figure 5 is encouraging, but the gate’s reliability across benchmarks and training stages remains unclear.

Q1: How often does a positive utility score select a skill that actually reduces downstream success? A breakdown by Scout outcome group and training stage would help assess whether the zero threshold is reliable.

Response: Thanks for the question and suggestion. We agree that making observed failures less likely does not by itself guarantee successful behavior. We therefore evaluate the positive-utility selections against fresh downstream outcomes across all Scout outcome groups (all-success, all-failure, and mixed) at different training stages.

Evaluation Setup. We evaluate checkpoints at steps 25/50/75 (ALFWorld) and 50/100/150 (WebShop). For each selected skill, we freeze the policy and run 8 fresh rollouts with and without the skill on the same query. Decline Rate denotes the fraction of selected queries where the skill-guided success rate is lower than the skill-free baseline (i.e., indicating negative transfer).

ALFWorld

CheckpointScout GroupSelected / TotalSkill-free SR (%)Skill-guided SR (%)Δ (pp)Decline Rate
Early (25)All-success0 / 50N/AN/AN/AN/A
All-failure28 / 2814.2917.86+3.574/28 (14.29%)
Mixed8 / 567.816.25−1.562/8 (25.00%)
Mid (50)All-success0 / 75N/AN/AN/AN/A
All-failure13 / 1326.9225.00−1.923/13 (23.08%)
Mixed2 / 4612.5018.75+6.251/2 (50.00%)
Late (75)All-success0 / 98N/AN/AN/AN/A
All-failure7 / 714.2921.43+7.141/7 (14.29%)
Mixed1 / 290.0025.00+25.000/1 (0.00%)

WebShop

CheckpointScout GroupSelected / TotalSkill-free SR (%)Skill-guided SR (%)Δ (pp)Decline Rate
Early (50)All-success2 / 201100.00100.000.000/2 (0.00%)
All-failure0 / 406N/AN/AN/AN/A
Mixed0 / 54N/AN/AN/AN/A
Mid (100)All-success32 / 20094.1491.80−2.347/32 (21.88%)
All-failure0 / 378N/AN/AN/AN/A
Mixed6 / 8347.9268.75+20.831/6 (16.67%)
Late (150)All-success35 / 26398.2197.50−0.712/35 (5.71%)
All-failure0 / 350N/AN/AN/AN/A
Mixed3 / 4850.0091.67+41.670/3 (0.00%)
  1. Guidance from Failed Scouts Across Stages: Even when all Scouts fail, our utility score can extract beneficial guidance at early and late checkpoints (+3.57 pp / +7.14 pp on ALFWorld), showing that the metric can learn from failed trajectories.
  2. Limited Observed Negative Transfer: Across all groups, the vast majority of selections maintain or improve performance. While some small subsets show empirical decline rates up to 50% (1/2), the overall pooled decline rates remain 12.8% on WebShop and 18.6% on ALFWorld.
  3. Effective Guidance on Challenging Tasks: Under the zero threshold, selected skills yield positive pooled average gains (+2.5 pp / +1.9 pp on ALFWorld/WebShop). Notably, on WebShop’s challenging mixed-difficulty cohorts, selected skills yield substantial downstream boosts in mid-to-late stages (e.g., +20.83 pp and +41.67 pp), supporting the utility metric’s ability to target ambiguous or non-trivial queries effectively as training progresses.

The protocol and full results are now in Appendix B.9 of the revised manuscript.

AuthorsOpenReview ↗

Reply to Reviewer Xz25(2/4)

(2) W2 & Q2: Training Cost and Efficiency Comparison

W2: The overall training-cost advantage is unclear. Candidate generation and trajectory rescoring add computation, but the paper does not report actual training time or comparisons under the same compute budget.

Q2: Were the RL baselines matched to SkillScaffold in environment interactions? What is the measured training overhead from candidate generation and trajectory scoring, and how do the methods compare at the same total compute budget?

Response: We thank the reviewer for the questions on training costs and budget matching. Yes, the RL baselines are strictly matched to SkillScaffold in total environment interactions (using G=8G=8 trajectories per query). To provide a complete picture, we break down the theoretical overhead, report measured wall-clock runtimes, and compare total budgets across baselines.

1. Theoretical Cost & Pipeline Breakdown

With N=L=4N=L=4, SkillScaffold partitions the Executor's rollout budget into two sequential stages per query—Scout rollouts (N=4N=4) followed by Post-Scout rollouts (L=4L=4)—matching standard GRPO's total trajectory budget (G=N+L=8G = N + L = 8). Between these two stages, candidate evaluation requires zero extra environment rollouts, relying strictly on teacher-forcing forward passes over existing Scout trajectories. Reusing skill-free scores, the maximum forward scorings per query (N=M=4N=M=4) are Kgroup=N(M+1)=20K_{\mathrm{group}} = N(M+1) = 20 and Kanchor=M+1=5K_{\mathrm{anchor}} = M+1 = 5. Consequently, the total compute difference relative to plain GRPO is ΔC=Cskill gen+Cscoring+CGenerator update+ΔCExecutor\Delta C = C_{\mathrm{skill\,gen}} + C_{\mathrm{scoring}} + C_{\mathrm{Generator\,update}} + \Delta C_{\mathrm{Executor}} (where CGenerator updateC_{\mathrm{Generator\,update}} denotes the Generator's GRPO gradient step, and ΔCExecutor\Delta C_{\mathrm{Executor}} captures shifts from skill-context prefixes and trajectory lengths).

2. Measured Per-Step Runtime & Asynchronous Execution

For Qwen3-8B (batch size 16), average per-step wall-clock timings break down into two main components—the rollout & scaffolding phase and the policy update phase:

Per-Step Timing Breakdown (s)ALFWorldWebShop
1. Rollout & Scaffolding Phase (Subtotal)190.165.4
├── Scout rollout75.730.6
├── Skill generation5.80.9
├── Utility scoring6.30.5
└── Post-Scout rollout102.333.4
2. Policy Update Phase69.130.2
└── Log-prob recomputation & Actor/Generator updates69.130.2
Complete Step (incl. async overhead & waiting)322.7149.0

As shown above, the primary scaffolding operations—skill generation (5.8 s / 0.9 s) and utility scoring (6.3 s / 0.5 s)—account for 3.75% (12.1 s) of total step time on ALFWorld and 0.94% (1.4 s) on WebShop. The remaining terms in ΔC\Delta C are similarly bounded: ΔCExecutor\Delta C_{\mathrm{Executor}} is reflected in the modest difference between Post-Scout and Scout rollout times (102.3s vs. 75.7s on ALFWorld) due to skill-context prefixes, while CGenerator updateC_{\mathrm{Generator\,update}} is amortized within the Policy Update Phase (69.1s / 30.2s).

Moreover, queries run through an asynchronous pipeline without batch-wide barriers between rollout stages: once a query’s four Scouts finish, it proceeds to skill generation and scoring and enqueues its Post-Scout rollouts subject to shared concurrency limits. Different queries can therefore occupy different stages concurrently, overlapping execution across the shared rollout and environment worker pools.

AuthorsOpenReview ↗

Reply to Reviewer Xz25(3/4)

3. Wall-Clock & Budget Comparison Across Baselines

To address the matched-budget concern, we compare total training costs under an identical 8×H1008 \times \text{H100} setup:

MethodExtra Stages / Memory BankSFT CostALFWorld CostWebShop CostPrimary Extra Overhead
GRPONone—5×85 \times 8 h4×84 \times 8 h—
SkillRLSFT + Bank + Teacher0.27×80.27 \times 8 h7×87 \times 8 h7×87 \times 8 hUpstream SFT & external teacher APIs
Skill-1Bank—12×812 \times 8 h10×810 \times 8 hRetrieval, reranking & bank maintenance
Evolving-RLTask Retriever—10×810 \times 8 h9×89 \times 8 hTask retrieval & downstream rollouts
SkillScaffoldNone (Online)—10×810 \times 8 h8×88 \times 8 hOnline skill gen., scoring & Generator update
  • Favorable Matched-Budget Efficiency vs. Skill-1 & Evolving-RL: SkillScaffold achieves superior performance while reducing RL wall-clock hours from 12×812 \times 8 h down to 10×810 \times 8 h on ALFWorld (a 16.7% reduction) and from 10×810 \times 8 h down to 8×88 \times 8 h on WebShop (a 20.0% reduction) compared to Skill-1, and matches or beats Evolving-RL (9×89 \times 8 h vs. 8×88 \times 8 h, 11.1% faster on WebShop). Unlike Skill-1 (which incurs heavy query generation, embedding retrieval/reranking, and persistent library pruning) and Evolving-RL (which requires task retrieval and extra downstream rollouts), SkillScaffold scores existing Scouts directly without a persistent bank.
  • Competitive Total Cost vs. SkillRL: While SkillRL reports slightly fewer RL hours (7×87 \times 8 h), it requires an additional upstream SFT stage (0.27×80.27 \times 8 h) plus continuous teacher-model intervention for skill distillation and bank evolution, incurring substantial unquantified external API costs.

Overall, under matched or lower resource budgets, SkillScaffold provides highly competitive training efficiency among skill-based RL methods without relying on persistent memory banks, external retrievers, or teacher APIs. We have added the training-cost comparison to Table 6 in the main text and the detailed runtime breakdown to Appendix B.8 of the revised manuscript.


AuthorsOpenReview ↗

Reply to Reviewer Xz25(4/4)

(3) W3 & Q3: Skill-Free Resampling Control for Figure 6

W3: The mechanism analyses need better controls. In Figure 6, fresh samples could recover from all-wrong Scouts even without skills.

Q3 (Figure 6): For Figure 6, how much recovery occurs with four fresh skill-free rollouts on the same all-wrong queries and frozen policy?

Response: Thanks for suggesting this control. The all-failure ALFWorld groups in our additional evaluation provide this comparison. At each checkpoint, we freeze the policy and collect eight fresh skill-free and eight skill-guided rollouts on the same all-wrong queries. All queries in these groups pass the gate, so the comparison covers the entire all-wrong group at each checkpoint.

CheckpointQueriesFresh skill-free SR (%)Fresh skill-guided SR (%)Δ (pp)
Early (step 25)2814.2917.86+3.57
Middle (step 50)1326.9225.00−1.92
Late (step 75)714.2921.43+7.14

Fresh skill-free rollouts recover 14.29%–26.92% success despite the original Scouts all failing. Compared with this baseline, skill guidance provides additional gains at the early and late checkpoints.

We acknowledge that our original discussion of Figure 6 did not sufficiently disentangle sampling variability from the contribution of skill guidance. We therefore qualify our interpretation in revised Section 5.5, clarifying that the observed Post-Scout improvements reflect the combined effects of stochastic recovery from fresh sampling and skill guidance, rather than the contribution of skills alone.


(4) W3 & Q3: No-Executor-Injection Control for Table 4

W3: Similarly, the later gains in Table 4 could partly reflect ordinary RL progress rather than skill internalization.

Q3 (Table 4): For Table 4, how does recovery on the same fixed cohorts compare with the no-Executor-injection variant?

Response: Thanks for the question and suggestion. We agree that early-to-late improvement alone does not isolate the contribution of skill-guided training. We therefore add a controlled continuation experiment on WebShop and ALFWorld.

We retain the same fixed cohorts from Table 4 and fork the same early checkpoint into two branches: Full SkillScaffold and a no-Executor-injection variant. The latter retains Generator learning and environment-reward-based Executor training, but disables skill injection during subsequent training. Both branches are evaluated without skills.

BenchmarkNSkillScaffold SRNo-injection SRDifference (pp)
WebShop1934.90%29.60%+5.3
ALFWorld5449.50%46.30%+3.2

Because both branches start from the same early policy, these late-stage differences also equal their differences in early-to-late recovery. Combining this comparison with Table 4, recovery is +19.7 vs. +14.4 pp on WebShop and +29.6 vs. +26.4 pp on ALFWorld for Full versus no injection.

Thus, continued training accounts for part of the recovery, while Executor skill injection provides an additional 5.3/3.2 pp improvement on WebShop/ALFWorld that remains available under skill-free evaluation.


Thank you again for these suggestions, which helped us strengthen utility validation, clarify training costs, and better isolate the contribution of skill guidance.

Reviewer_yFyyOpenReview ↗
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Paper summary

SkillScaffold uses generated textual skills as temporary guidance during agentic reinforcement learning. A shared policy first collects skill-free trajectories, then generates candidate skills from their outcomes. Candidates are scored by how they change the likelihood of successful and failed trajectories, and the highest-scoring skill is injected only when its estimated utility is positive. The same policy learns both skill generation and task execution, while deployment uses no external skills. Experiments on ALFWorld, WebShop, ScienceWorld, and τ²-Bench report improvements over standard RL and several skill-based methods.

Critical strengths

The method produces consistent improvements, and the component ablations are useful. SkillScaffold reaches 45.1 on WebShop and 94.8 on ALFWorld, compared with 41.8 and 91.8 for the strongest listed competitors, while operating without skills at inference. Table 3 examines generator learning, candidate selection, abstention, and skill injection, with performance decreasing when these components are removed or disrupted. Section 5.4 also evaluates the utility score using separate downstream rollouts. Together, these experiments provide reasonable evidence that the proposed combination is useful.

Critical weaknesses
  1. The methodological advance appears relatively narrow. As the introduction acknowledges, generating guidance from experience, jointly improving skill generation and execution, and training toward skill-free deployment are established directions. The main distinct contribution here is the outcome-aware likelihood score and its use for selection, abstention, and generator supervision. This is a sensible design, but I am not yet convinced that it represents a substantial advance over existing adaptive scaffolding approaches. The ablations establish that the components matter within this system; comparisons against random selection, shuffled utilities, and unconditional injection provide less evidence that the proposed score offers an advantage over simpler, plausible alternatives. For example, a gate based on Scout success rate would help distinguish the value of the new estimator from the benefit of selectively assisting difficult queries.

  2. The empirical evidence does not yet make the practical significance of this incremental contribution compelling. The main tables report point estimates without uncertainty across training runs. Since several gains over strong competitors are around 3–4 percentage points, their reliability matters to the assessment. The efficiency argument also rests mainly on avoiding candidate-specific environment rollouts. Skill generation and repeated trajectory scoring still incur computation, and the paper does not report measured training costs or clearly establish comparisons under matched total budgets. These gaps leave uncertainty about whether the additional machinery offers a robust and practically meaningful improvement.

Questions for authors
  1. Evidence for the contribution: How does the proposed utility-based selection compare with a simpler policy that injects guidance according to Scout success rate or another measure of task difficulty? This would help isolate the benefit of the likelihood-based estimator.

  2. Clarification of experimental reliability: How many independent training runs underlie Tables 1–3, and what is the variation across runs? In particular, are the improvements over the strongest skill-based baselines consistent?

  3. Evidence for the efficiency claim: What are the total training costs, including skill generation and trajectory rescoring, relative to the strongest baselines? Does the performance advantage remain under a matched compute or wall-clock budget?

4 comments
AuthorsOpenReview ↗

Reply to Reviewer yFyy(1/4)

Thank you for your careful review and constructive suggestions!

Summary. Your main concerns are the methodological contribution beyond existing adaptive scaffolding, the benefit over simpler difficulty-based injection, cross-run reliability, and total training efficiency. Below, we clarify our contribution, present Scout-success-based controls and three-seed comparisons against the strongest baselines, and report measured training costs and budget comparisons.


(1) W1: Clarifying Methodological Novelty and Advances

W1: The methodological advance appears relatively narrow. As the introduction acknowledges, generating guidance from experience, jointly improving skill generation and execution, and training toward skill-free deployment are established directions. The main distinct contribution here is the outcome-aware likelihood score and its use for selection, abstention, and generator supervision. This is a sensible design, but I am not yet convinced that it represents a substantial advance over existing adaptive scaffolding approaches.

Response: We fully agree that generating skill guidance, joint skill improvement, and skill-free deployment are established macro-directions in skill-based RL, as explicitly acknowledged in our introduction. However, we respectfully argue that SkillScaffold introduces substantive novelty and fundamental advances by addressing a critical missing piece that prior works gloss over: Skill Credit Assignment under a training-time scaffold view.

Existing adaptive scaffolding methods fail to provide an efficient and accurate credit signal, falling into three flawed paradigms:

  1. Blind Injection (e.g., SkillRL): Assumes all generated skills are beneficial and injects them unconditionally. As shown in our Figure 3b, this causes severe negative transfer once the policy becomes competent on a query.
  2. Delayed and Indirect Feedback (e.g., Skill1): Assigning credit based on a skill’s success rate on historical tasks for which it was retrieved. Such aggregated feedback may lag behind policy updates and does not directly measure the candidate’s utility for the current policy and query.
  3. Rollout-Based Evaluation (e.g., Evolving-RL): Estimating skill utility through environment rollouts on downstream tasks where the skill is retrieved. However, reliable estimates require many samples, incurring substantial interaction costs (Figure 2).

Rather than serving as a minor scoring heuristic, our outcome-aware likelihood utility establishes a principled training-time scaffolding paradigm that unifies three tightly coupled mechanisms under a single signal:

  1. Selective Scaffolding via Abstention (Whether to Inject): Unlike existing methods that inject skills unconditionally, our positive-gated rule dynamically decides whether guidance is needed—actively abstaining and discarding all candidates to prevent negative transfer when the current policy is already competent on a query or when generated skills are unhelpful.
  2. Rollout-Free, Policy-Relative Credit Assignment (Which Skill to Inject): To identify the optimal candidate, SkillScaffold scores all generated skills by computing likelihood shifts over existing outcome-verified Scout trajectories—obtaining a direct, policy-relative credit signal with zero extra environment rollouts.
  3. Co-Adaptive Generator Supervision (Evolving with the Executor): Because utility is computed relative to the current Executor's trajectories, reusing this exact score as dense GRPO supervision drives the Generator to continuously adapt its generated skills as the Executor improves over training.

Together, this unified utility signal seamlessly couples abstention, selection, and co-evolution into an efficient, self-adaptive training scaffold.


AuthorsOpenReview ↗

Reply to Reviewer yFyy(2/4)

(2) W1 & Q1: Ablation Study on Scout-Success-Based Skill Injection

W1: The ablations establish that the components matter within this system; comparisons against random selection, shuffled utilities, and unconditional injection provide less evidence that the proposed score offers an advantage over simpler, plausible alternatives. For example, a gate based on Scout success rate would help distinguish the value of the new estimator from the benefit of selectively assisting difficult queries.

Q1: 1. Evidence for the contribution: How does the proposed utility-based selection compare with a simpler policy that injects guidance according to Scout success rate or another measure of task difficulty? This would help isolate the benefit of the likelihood-based estimator.

Response: Thanks for the question and suggestion. Following your suggestion, we add two controlled ablations to examine utility-based selection more closely. All other components, including Generator learning, remain unchanged.

  • Scout-success gate (Variant A): We replace the positive-utility gate with a Scout-success gate: guidance is injected when the mean Scout reward is below 0.5. When injection is triggered, we retain the utility-ranked top-1 skill. Comparing A with SkillScaffold isolates the contribution of utility-based gating.
  • Scout-success gate & random selection (Variant B): Starting from A, we additionally replace utility-ranked selection with random selection among valid candidates. Comparing B with SkillScaffold examines the combined contribution of utility-based gating and candidate ranking. Comparing A with B further isolates the contribution of utility-based candidate ranking under the same Scout-success gate.
MethodALFWorldWebShop
SkillScaffold (Full)94.845.1
w/ Scout-success gate90.0440.39
w/ Scout-success gate & random selection88.2839.60

SkillScaffold outperforms A by 4.76/4.71 percentage points on ALFWorld/WebShop, supporting utility-based gating beyond selectively assisting difficult queries. Replacing candidate ranking with random selection further decreases performance by 1.76/0.79 points. Overall, SkillScaffold exceeds B by 6.52/5.50 points, providing evidence that candidate-specific utility contributes through both injection decisions and candidate selection.


(3) W2 & Q2: Reliability across Multi-Seed training runs

 W2: The empirical evidence does not yet make the practical significance of this incremental contribution compelling. The main tables report point estimates without uncertainty across training runs. Since several gains over strong competitors are around 3–4 percentage points, their reliability matters to the assessment.

Q2: Clarification of experimental reliability: How many independent training runs underlie Tables 1–3, and what is the variation across runs? In particular, are the improvements over the strongest skill-based baselines consistent?

Response: We fully agree that reporting uncertainty across training runs is crucial for establishing the practical significance of these performance gains.

Regarding Tables 1–3 in the original submission, the reported numbers reflect results from single training runs (evaluated via pass@1 averaged over k=8k=8 rollouts per task), as full-scale multi-seed RL training at this scale is computationally intensive. To directly address your concern and verify consistency, we reran SkillScaffold and the strongest skill-based RL baselines—SKILL1 on ALFWorld and Evolving-RL on WebShop—across three independent random seeds. The mean ± standard deviation results are reported below:

BenchmarkMethodSuccess rate (%)
ALFWorldSkillScaffold*93.94 ± 0.74
ALFWorldSKILL1†90.30 ± 1.37
WebShopSkillScaffold*45.04 ± 1.30
WebShopEvolving-RL†40.60 ± 1.17
(* denotes skill-free evaluation; † denotes evaluation with skills.)

Across independent runs, SkillScaffold maintains a clear performance margin over the strongest baselines—surpassing SKILL1 by 3.64 pp on ALFWorld and Evolving-RL by 4.44 pp on WebShop with tight standard deviations. These multi-seed evaluations firmly validate the reliability and robustness of our approach.


AuthorsOpenReview ↗

Reply to Reviewer yFyy(3/4)

(4) W2 & Q3: Training Cost and Efficiency Comparison

W2: The efficiency argument also rests mainly on avoiding candidate-specific environment rollouts. Skill generation and repeated trajectory scoring still incur computation, and the paper does not report measured training costs or clearly establish comparisons under matched total budgets. These gaps leave uncertainty about whether the additional machinery offers a robust and practically meaningful improvement.

Q3: Evidence for the efficiency claim: What are the total training costs, including skill generation and trajectory rescoring, relative to the strongest baselines? Does the performance advantage remain under a matched compute or wall-clock budget?

Response: We thank the reviewer for highlighting the need to quantify total training costs and compare under matched budgets. We break down the theoretical overhead, report measured wall-clock runtimes, and compare total budgets across baselines.

1. Theoretical Cost & Pipeline Breakdown

With N=L=4N=L=4, SkillScaffold partitions the Executor's rollout budget into two sequential stages per query—Scout rollouts (N=4N=4) followed by Post-Scout rollouts (L=4L=4)—matching standard GRPO's total trajectory budget (G=N+L=8G = N + L = 8). Between these two stages, candidate evaluation requires zero extra environment rollouts, relying strictly on teacher-forcing forward passes over existing Scout trajectories. Reusing skill-free scores, the maximum forward scorings per query (N=M=4N=M=4) are Kgroup=N(M+1)=20K_{\mathrm{group}} = N(M+1) = 20 and Kanchor=M+1=5K_{\mathrm{anchor}} = M+1 = 5. Consequently, the total compute difference relative to plain GRPO is ΔC=Cskill gen+Cscoring+CGenerator update+ΔCExecutor\Delta C = C_{\mathrm{skill\,gen}} + C_{\mathrm{scoring}} + C_{\mathrm{Generator\,update}} + \Delta C_{\mathrm{Executor}} (where CGenerator updateC_{\mathrm{Generator\,update}} denotes the Generator's GRPO gradient step, and ΔCExecutor\Delta C_{\mathrm{Executor}} captures shifts from skill-context prefixes and trajectory lengths).

2. Measured Per-Step Runtime & Asynchronous Execution

For Qwen3-8B (batch size 16), average per-step wall-clock timings break down into two main components—the rollout & scaffolding phase and the policy update phase:

Per-Step Timing Breakdown (s)ALFWorldWebShop
1. Rollout & Scaffolding Phase (Subtotal)190.165.4
├── Scout rollout75.730.6
├── Skill generation5.80.9
├── Utility scoring6.30.5
└── Post-Scout rollout102.333.4
2. Policy Update Phase69.130.2
└── Log-prob recomputation & Actor/Generator updates69.130.2
Complete Step (incl. async overhead & waiting)322.7149.0

As shown above, the primary scaffolding operations—skill generation (5.8 s / 0.9 s) and utility scoring (6.3 s / 0.5 s)—account for 3.75% (12.1 s) of total step time on ALFWorld and 0.94% (1.4 s) on WebShop. The remaining terms in ΔC\Delta C are similarly bounded: ΔCExecutor\Delta C_{\mathrm{Executor}} is reflected in the modest difference between Post-Scout and Scout rollout times (102.3s vs. 75.7s on ALFWorld) due to skill-context prefixes, while CGenerator updateC_{\mathrm{Generator\,update}} is amortized within the Policy Update Phase (69.1s / 30.2s).

Moreover, queries run through an asynchronous pipeline without batch-wide barriers between rollout stages: once a query’s four Scouts finish, it proceeds to skill generation and scoring and enqueues its Post-Scout rollouts subject to shared concurrency limits. Different queries can therefore occupy different stages concurrently, overlapping execution across the shared rollout and environment worker pools.

AuthorsOpenReview ↗

Reply to Reviewer yFyy(4/4)

3. Wall-Clock & Budget Comparison Across Baselines

To address the matched-budget concern, we compare total training costs under an identical 8×H1008 \times \text{H100} setup:

MethodExtra Stages / Memory BankSFT CostALFWorld CostWebShop CostPrimary Extra Overhead
GRPONone—5×85 \times 8 h4×84 \times 8 h—
SkillRLSFT + Bank + Teacher0.27×80.27 \times 8 h7×87 \times 8 h7×87 \times 8 hUpstream SFT & external teacher APIs
Skill-1Bank—12×812 \times 8 h10×810 \times 8 hRetrieval, reranking & bank maintenance
Evolving-RLTask Retriever—10×810 \times 8 h9×89 \times 8 hTask retrieval & downstream rollouts
SkillScaffoldNone (Online)—10×810 \times 8 h8×88 \times 8 hOnline skill gen., scoring & Generator update
  • Favorable Matched-Budget Efficiency vs. Skill-1 & Evolving-RL: SkillScaffold achieves superior performance while reducing RL wall-clock hours from 12×812 \times 8 h down to 10×810 \times 8 h on ALFWorld (a 16.7% reduction) and from 10×810 \times 8 h down to 8×88 \times 8 h on WebShop (a 20.0% reduction) compared to Skill-1, and matches or beats Evolving-RL (9×89 \times 8 h vs. 8×88 \times 8 h, 11.1% faster on WebShop). Unlike Skill-1 (which incurs heavy query generation, embedding retrieval/reranking, and persistent library pruning) and Evolving-RL (which requires task retrieval and extra downstream rollouts), SkillScaffold scores existing Scouts directly without a persistent bank.
  • Competitive Total Cost vs. SkillRL: While SkillRL reports slightly fewer RL hours (7×87 \times 8 h), it requires an additional upstream SFT stage (0.27×80.27 \times 8 h) plus continuous teacher-model intervention for skill distillation and bank evolution, incurring substantial unquantified external API costs.

Overall, under matched or lower resource budgets, SkillScaffold provides highly competitive training efficiency among skill-based RL methods without relying on persistent memory banks, external retrievers, or teacher APIs. We have added the training-cost comparison to Table 6 in the main text and the detailed runtime breakdown to Appendix B.8 of the revised manuscript.


Thank you again for your constructive suggestions, which motivated additional ablations to isolate the benefit of the likelihood-based estimator, multi-seed evaluations to strengthen evidence for reliability, and training-cost analysis to clarify practical efficiency.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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