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Under review as a conference paper at ICLR 2027

Beyond Correctness: Learning Robust Reasoning via Transfer

Abstract

Reinforcement Learning with Verifiable Rewards (RLVR) has recently strengthened LLM reasoning, but its focus on final-answer correctness leaves a critical gap: equally correct solutions can differ in the usefulness of their intermediate reasoning. We adopt a simple philosophical view—good reasoning should remain useful beyond the mind that produced it—and treat reasoning as a form of meaning transfer that can be assessed through truncation and continuation by another model. Building on this principle, we introduce Reinforcement Learning with Transferable Reward (RLTR), which rewards reasoning prefixes that support correct continuation by a separate model. This objective turns the usefulness of intermediate reasoning to another model into an auxiliary training signal for improving the generator itself. Our approach improves majority-vote accuracy while improving final-answer accuracy, and it reaches comparable performance in substantially fewer training steps. For example, RLTR gains a +5.8%p in Maj@64 on AMC23 compared to RLVR, and RLTR matches RLVR’s average accuracy with roughly 2.5× fewer training steps on MATH-500. Extensive analyses further support RLTR’s effectiveness, showing improved prefix utility for held-out receivers.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Large Language Model, Reinforcement Learning, RLVR, Process

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_8b7nOpenReview ↗
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3
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Paper summary

This paper proposes Reinforcement Learning with Transferable Reward (RLTR), which augments outcome-based reinforcement learning with feedback from another model’s continuation of a reasoning prefix. The generator first produces a complete solution. A randomly retained fraction of its reasoning, excluding the terminal answer span, is then supplied to a frozen receiver. The correctness of one sampled receiver continuation provides an auxiliary reward, which is combined with the generator’s answer and format rewards to train the generator using GRPO. The method does not require training a separate process reward model. The principal evaluation uses a Qwen2.5-7B-Instruct generator and a Qwen2.5-3B-Instruct receiver, with additional experiments on stronger language models, another model family, and vision-language reasoning. The paper reports improvements in average accuracy and majority-vote accuracy, reduced training cost to reach a target accuracy, and improved prefix utility for held-out receivers. It also compares against process-reward, frozen self-continuation, and MRT-style progress baselines.

Critical strengths
  1. A simple training modification produces practically relevant performance and efficiency gains. RLTR adds a directly verifiable auxiliary signal without requiring a separately trained process reward model. The reported improvements are not restricted to the receiver-continuation metric being optimized: the generator itself improves. For example, Table 11 reports MATH-500 average accuracy increasing from 76.2 to 77.0 and Maj@64 from 82.2 to 84.2 relative to RLVR; AMC23 Maj@64 increases from 61.7 to 67.5. The Qwen3 and Llama experiments provide additional evidence that the effect is not specific to the main generator checkpoint. These results make the method potentially useful as a relatively simple addition to an existing RL training pipeline.
    Importantly, the efficiency evidence goes beyond counting optimization steps. Table 2 reports reaching 76.2% MATH-500 accuracy in 2.4 hours with RLTR versus 4.8 hours with RLVR, while explicitly including the additional receiver computation in the comparison. This is a consequential practical result, although the precise FLOP accounting would benefit from the clarification requested below.

  2. The paper includes meaningful controls for several obvious alternative explanations. The experimental design is substantially stronger than a comparison against outcome-only RL alone. Appendix A.3 specifies three training seeds and checkpoint selection on a separate validation set, without using test performance for selection. Appendix B.6 includes both frozen self-continuation and a progress-based control, as well as a reward-assignment control that permutes transfer rewards among responses to the same problem. The latter is especially useful because it tests whether assigning receiver feedback to the particular response that produced it matters, rather than merely reproducing the within-group distribution of auxiliary rewards.
    The held-out receiver evaluation also includes question-only, shuffled-prefix, and answer-masked conditions. In Table 9, the masked RLTR–RLVR differences remain positive with confidence intervals excluding zero at truncation ratios 0.3 and 0.5. This provides evidence that the observed advantage is not explained solely by the explicit answer spans removed by the masking procedure. These controls materially strengthen the empirical case for useful prefix-dependent supervision.

Critical weaknesses
  1. The distinctive contribution and the attribution to “cross-model transfer” remain only partly isolated. In expectation, the transfer reward estimates a frozen receiver’s probability of successful continuation from a prefix. The broader idea of improving a policy using another, potentially weaker, prover’s assessment of intermediate progress already appears in Rewarding Progress / PAV. That work explicitly emphasizes complementary prover policies distinct from the base policy. RLTR’s meaningful distinction is therefore its direct online continuation feedback, random-prefix construction, and avoidance of a learned process verifier—not the use of another model’s reasoning ability by itself. The submission acknowledges this related work, but the conceptual contribution should remain scoped accordingly. The receiver comparisons do not fully resolve this distinction. RLTR-self uses a frozen copy of the initial 7B generator, rather than the current policy, while the main method uses a separately pretrained 3B receiver. This changes receiver capacity and continuation behavior as well as its relationship to the generator. The MRT-based control also uses the frozen initial-policy prover and changes the reward construction and credit assignment. Consequently, Table 11 demonstrates that the selected RLTR configuration performs well, but does not cleanly establish whether the decisive factor is cross-model transfer, a better-calibrated receiver, or the particular auxiliary-reward construction. A progress-based comparison using the same 3B receiver would be especially informative. This limits the strength of the claimed mechanistic contribution, although it does not negate the practical results.
  2. Relative-length truncation leaves an important token-budget confound in the interpretation of prefix utility. The retained prefix length is defined as a fraction of the generator’s completed reasoning length. Thus, the same truncation ratio does not necessarily expose the receiver to the same number of tokens across methods. Longer generated solutions could supply longer prefixes at every ratio, potentially improving continuation accuracy without improving the usefulness of reasoning at a fixed token budget. Because the boundary depends on the completed trace length, this is relevant to both the evaluation and the incentives induced during training. The manuscript does not report the corresponding trace-length distributions or fixed-absolute-prefix-length comparisons. This is a possible alternative explanation, not evidence that the model actually exploits it.
    The existing masking and shuffled-prefix controls are valuable, but address different questions. Moreover, the held-out gains are not uniformly decisive: for the Llama receiver, the genuine-prefix differences at ratios 0.5 and 0.7 are +0.73 and +0.27 percentage points, with both confidence intervals including zero. The evidence therefore supports useful transfer in some conditions more strongly than a general improvement across interruption points. Reporting fixed-token comparisons, together with actual generator and receiver token counts, would substantially strengthen the reasoning-quality interpretation and help validate the precise computational-overhead estimates. Table 8 currently assigns identical generator-side FLOPs to the two methods, making the assumptions behind this accounting particularly relevant.
Questions for authors
  1. Please report the generator reasoning-length and retained-prefix-length distributions for RLVR and RLTR. Can the held-out continuation comparison be repeated at fixed absolute prefix lengths, with matched receiver continuation budgets? This would help distinguish improved prefix usefulness from providing the receiver with more generated context. A correctness-stratified comparison would additionally help separate prefix quality from differences in the frequency of successful generator solutions.
  2. The self-continuation and MRT-based controls use the frozen initial 7B policy, whereas RLTR uses the 3B receiver. How does an MRT-style progress reward perform when estimated using the same frozen 3B receiver under a comparable continuation budget? Such a comparison would materially affect my assessment of whether the contribution is principally the receiver choice or the transfer-reward construction. Please also distinguish conclusions about frozen initial-policy continuation from conclusions about continuation by the current policy.
  3. Are the FLOPs in Tables 2 and 8 computed from actual executed sequence lengths, padded lengths, or configured maximum lengths? Does the receiver rollout cost include processing the question and transferred prefix as well as generating the continuation? Please explain the identical generator-side costs in Table 8 and clarify whether the wall-clock measurements use identical hardware allocations and include all method-specific training operations. The wall-clock result is already useful; these details would determine how strongly I interpret the reported approximately 7% FLOP overhead and its likely generality.
5 comments
AuthorsOpenReview ↗

Response to Reviewer 8b7n (1/3)

Thank you for the detailed assessment. We added the same-receiver progress control, fixed-prefix-length and correctness-stratified evaluations, and a corrected account of our compute estimates.


[W1 & Q2] Receiver choice or transfer-reward construction? Relation to PAV and MRT

The same-receiver control shows that receiver identity alone does not explain the advantage of the evaluated RLTR configuration.

The generator is rewarded with the checked outcome of one fresh continuation, by a separate frozen receiver, from a randomly truncated prefix of its current reasoning. This adds a process-level signal to RLVR at the cost of one extra rollout: no learned process verifier is trained or queried, and no step segmentation or progress differences are computed. It improves the generator's own accuracy and Maj@K, keeps Pass@64 close to the base model's level where RLVR lowers it (95.0 vs. 92.2 on MATH-500), and halves the wall-clock time to RLVR's accuracy (2.4 vs. 4.8 hours).

Relation to PAV and MRT. As you note, using a second model is not what is new. In your words, RLTR's distinction is its "direct online continuation feedback, random-prefix construction, and avoidance of a learned process verifier," and the revised contribution statement adopts this scope. PAV's RL pipeline rewards the policy through a fixed verifier trained on prover rollouts, not through fresh prover continuations [1]. MRT's open-ended implementation combines same-model thought-termination probes with continued reasoning to estimate progress [2], and its general formulation permits an external meta-prover. RLTR instead rewards one receiver continuation of a random prefix directly.

Receiver choice versus reward construction. We ran our MRT-style progress baseline with the same frozen Qwen2.5-3B receiver, as you suggested. Entries are Acc. / Maj@64 (%).

Method / frozen continuation modelAIME2024AMC23MATH-500GSM8K
MRT-based / initial 7B13.7 / 17.853.4 / 63.377.0 / 83.091.7 / 94.2
MRT-based / 3B (new)13.8 / 16.753.7 / 60.076.8 / 83.091.8 / 94.0
RLTR-self / initial 7B11.1 / 16.753.6 / 62.577.0 / 82.891.7 / 93.4
RLTR / 3B14.8 / 21.153.5 / 67.577.0 / 84.292.0 / 94.2

With the receiver fixed at 3B, RLTR has higher Maj@64 on all four benchmarks: +4.4 on AIME2024, +7.5 on AMC23, +1.2 on MATH-500, and +0.2 on GSM8K, where both methods are near saturation (94%). Accuracy is higher on three benchmarks and 0.2 lower on AMC23. We read this as an advantage for the evaluated RLTR configuration, not universal superiority of transfer over progress rewards; within that scope, moving the progress baseline to the 3B receiver does not reproduce RLTR's high-K performance.

Frozen initial policy versus current policy. Both 7B controls (RLTR-self and MRT-based / 7B) continue from a frozen copy of the initial generator, not from the updated policy. We draw no conclusion about continuation by the current policy, and Section 3.3 now makes this explicit.

Budget. The MRT-style control keeps Appendix B.6's segment-wise construction with two randomly placed boundaries, and the comparison fixes receiver identity while varying the truncation boundaries, reward construction, and credit assignment together. At each boundary, the continuation model is stopped from reasoning further (the thought block is closed with </think>) and gives its best-guess answer four times, for eight short generations per response (243 generated tokens each on average). RLTR uses one full continuation of one random prefix (433 generated tokens on average). The control therefore generates about 4.5 times as many receiver tokens per response as RLTR (1,944 vs. 433), before counting its eight-fold input processing, so RLTR's advantage does not come from a larger continuation budget.

References

[1] Amrith Setlur et al. Rewarding Progress: Scaling Automated Process Verifiers for LLM Reasoning. International Conference on Learning Representations, 2025.

[2] Yuxiao Qu et al. Optimizing Test-Time Compute via Meta Reinforcement Finetuning. International Conference on Machine Learning, 2025.

AuthorsOpenReview ↗

Response to Reviewer 8b7n (2/3)

[W2 & Q1] Is prefix utility explained by longer prefixes under relative-length truncation?

Longer prefixes alone do not explain the observed advantage: gains remain in several fixed-token conditions, including a held-out receiver at 100% coverage. At fixed absolute prefix lengths, every point estimate still favors RLTR, for both the training receiver and a held-out one. Nevertheless, your concern is well founded, because RLTR's solutions are longer on average. We therefore tested it directly, as you suggested.

Length statistics (MATH-500 evaluation outputs, Qwen2.5 tokens).

Token-length statisticRLVRRLTR
Mean generation length600694
Median generation length [P25, P75]485 [343, 752]481 [343, 786]
Mean retained prefix length at 30% / 50% / 70%180 / 300 / 419208 / 347 / 485

RLTR's mean length is 15.7% higher while the medians are similar.

Fixed prefix budgets. Each row uses the solution pairs eligible under both methods. Within each receiver, both methods share the same continuation cap, a maximum of 8,192 generated tokens. Prefix budgets are counted with the Qwen2.5 tokenizer for both receivers.

ReceiverPrefix tokensEligible n (coverage)RLVR (%)RLTR (%)RLTR − RLVR, pp [95% CI]
Qwen2.5-3B (training)1282,000 (100%)60.361.0+0.72 [−0.53, +2.00]
Qwen2.5-3B (training)2561,787 (89.3%)59.461.3+1.90 [+0.40, +3.43]
Qwen2.5-3B (training)3841,213 (60.6%)50.353.1+2.86 [+0.91, +4.78]
Llama-3.1-8B (held-out)1282,000 (100%)33.335.1+1.80 [+0.38, +3.20]
Llama-3.1-8B (held-out)2561,787 (89.3%)35.036.4+1.46 [−0.28, +3.21]
Llama-3.1-8B (held-out)3841,213 (60.6%)29.830.8+0.93 [−0.89, +2.76]

Intervals exclude zero for the training receiver at 256 and 384 tokens, and for the held-out receiver at 128 tokens, where coverage is 100%. The other three differences are positive but inconclusive, and we do not claim a gain in every condition. Eligibility changes with the budget, so comparisons are valid within rows, not across them.

Correctness-stratified comparison (training receiver, 256 tokens, same-problem solution pairs).

Original generator outcomesRLVR receiver acc. (%)RLTR receiver acc. (%)Difference, pp [95% CI]
Both correct78.380.1+1.73 [+0.11, +3.34]
Both incorrect7.48.8+1.47 [−0.64, +3.70]

Among pairs where both generators are correct, RLTR prefixes still help more. A higher rate of correct full solutions therefore cannot by itself explain the advantage within this subset. The both-incorrect difference is positive but inconclusive.

Separately, a blinded audit finds RLTR prefixes more often correct before any receiver continuation. On 2,400 prefixes from 100 MATH-500 problems, two LLM judges saw only the problem and the prefix. The difference is +4.2 pp [+1.0, +7.6] at 25% of the reasoning and +4.5 pp [+0.3, +9.0] at 50%; at 75% it is inconclusive (+2.8 pp [−1.7, +7.4]).

The revision states that prefix-utility gains depend on the receiver and the interruption point, rather than describing them as uniform.

AuthorsOpenReview ↗

Response to Reviewer 8b7n (3/3)

[Q3] How were FLOPs and wall-clock time computed?

The FLOPs in Tables 2 and 8 are analytical estimates at the configured maximum generation length (8,192 tokens), not executed or padded lengths. Both methods were assigned a 512-token prompt and this 8,192-token maximum, which is why the generator-side entries are identical. The receiver entry (66.49 PFLOPs) uses the same assumption and includes input processing.

Length sensitivity. Substituting the MATH-500 evaluation mean generation lengths (600 vs. 694 tokens) gives generator-side costs of 99.45 vs. 108.11 PFLOPs per step, an 8.7% increase. This sensitivity calculation uses different length assumptions from the 7.2% receiver-overhead estimate in Table 8, so the two estimates should be interpreted separately. The measured per-step wall-clock overhead is 25.2%, including receiver loading and unloading in verl and all other method-specific operations.

Executed lengths. The receiver's continuations averaged 433 generated tokens per response in training, far below the configured maximum. Run-wide FLOPs accounting would also require the generator's executed lengths during training and the corresponding padding and batching conventions.

Wall-clock. Our efficiency claim rests on measured time to the same accuracy: 76.2% on MATH-500 after 40 steps and 2.4 hours for RLTR, versus 100 steps and 4.8 hours for RLVR. All runs used the same hardware allocation, and the measurement includes every RLTR-specific operation, including loading and unloading the receiver in verl at each step.

Part of the per-step overhead (1.25× in the main setting, 1.53× with Qwen3) therefore reflects our implementation rather than receiver computation, and could be reduced with further engineering. We report the unoptimized figure. The revision separates analytical estimates, the length-sensitivity calculation, and measured wall-clock time.


How your review improved the paper. Your review led us to add the same-receiver progress control with its continuation budget (Section 3.3, Appendix E.2), fixed-prefix-length and correctness-stratified evaluations with length statistics (Appendix E.5), and a corrected account of our compute estimates (Appendix B.2), and to scope the contribution statement in your terms.

We hope the result and these additions address your concerns; if so, we would be grateful if you would consider updating your assessment.

Reviewer_WhQ3OpenReview ↗
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3
Confidence
2
Informativeness
2
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Paper summary

This paper proposes Reinforcement Learning with Transferable Reward (RLTR). A generator produces a complete solution, and a frozen receiver continues a randomly truncated reasoning prefix. The receiver's verified answer correctness provides an auxiliary reward alongside the generator's own correctness and format rewards. Experiments report improvements in average accuracy and majority-vote performance across language and vision-language models. Additional controls examine self-continuation, progress rewards, shuffled reward assignment, answer masking, unseen receivers, and training cost.

Critical strengths
  1. The idea is appealing and easy to implement. Rewarding the usefulness of intermediate reasoning to an external receiver provides a concrete way to encourage reasoning that others can reuse, without training a separate reward model.

  2. The empirical support is relatively broad, including multiple backbones, datasets, receiver controls, and three training seeds in the main setup. The AMC23 Maj@64 improvement from 61.7% to 67.5% is promising. The cost analysis also supports improved efficiency at a specific MATH-500 accuracy target.

Critical weaknesses
  1. The mechanism connecting transfer success to better reasoning remains unclear. A receiver may exploit correct intermediate information, adapt to a familiar presentation style, or correct errors and solve the problem again. The prefix controls provide useful evidence, but do not fully separate these explanations. Improvements in majority voting and receiver utility also do not by themselves establish greater logical correctness or robustness of the reasoning process.

  2. The incremental contribution and practical scope need clearer justification. PAV already studies progress under a distinct prover, and MRT permits an external meta-prover. The MRT-based control here changes both receiver choice and reward construction relative to RLTR, leaving their contributions partly confounded. Many single-sample gains are modest. The choice of a small receiver and the conditions under which its added computation remains worthwhile need more systematic analysis.

Questions for authors
  1. Can RLTR be compared with progress-based rewards using the same external receiver, truncation points, and total compute budget? This would help isolate its contribution beyond PAV/MRT-style continuation feedback.

  2. What evidence distinguishes useful reasoning content from presentation compatibility or receiver correction? Can controlled edits to key intermediate steps, with length and formatting held fixed, clarify the mechanism and test robustness?

  3. How should the receiver be selected? Please explain how receiver strength and model family affect reward discrimination, transfer to unseen receivers, and the accuracy-versus-compute trade-off as the generator becomes stronger.

3 comments
AuthorsOpenReview ↗

Response to Reviewer WhQ3 (1/3)

Thank you for the constructive review. We added the controlled prefix edits and the same-receiver progress comparison you proposed, and a direct correctness audit.


[W1 & Q2] Useful reasoning content, presentation compatibility, or receiver correction?

Receiver accuracy is sensitive to injected mathematical errors but changes little under the tested prose rewrites, and RLTR prefixes are more often correct before the receiver sees them. To test this directly, as you proposed, we compared each original prefix with a meaning-preserving presentation edit and with an edit that introduces a one-digit error in the most recent intermediate result.

The comparison uses the same frozen Qwen2.5-3B receiver, the same cut points, and the same continuation budget, across 12,757 paired prefix examples from both methods (452 questions). The presentation edit rewords only the English prose (Claude Haiku 5.5): every mathematical expression and number and the cut-off ending are kept verbatim, the line structure is unchanged, and lengths stay within 10% (mean ratio 1.00). A median of 31% of the prose words change, and Claude Opus 5.5 judged 196 of 200 random rewrites to keep the mathematical content unchanged.

Prefix condition (frozen Qwen2.5-3B receiver)Accuracy (%)Change from original, pp [95% CI]
Original prefix65.3Reference
Meaning-preserving presentation edit65.1−0.18 [−0.63, +0.26]
Substantive reasoning error introduced54.8−10.44 [−11.71, −9.24]

The tested prose rewrites have little effect (−0.18 pp), whereas a one-digit error in the latest derived value costs 10.4 points (difference between the two edits: +10.27 pp [+9.03, +11.54]), with the same pattern at every cut. Because the rewrite keeps the mathematical expressions and line structure, it does not test how the solution is organized. Split by method, RLTR's lead over RLVR is the same before and after the rewrite: +1.3 pp [+0.1, +2.4] on the original prefixes (66.0% vs. 64.7%) and +1.3 pp [+0.2, +2.5] on the rewritten ones (65.8% vs. 64.5%). The tested rewrites therefore do not remove RLTR's advantage.

The remaining 54.8% accuracy does not by itself distinguish correction of the injected error from use of unaffected earlier steps or solving the problem afresh. The paired 10.44-point decrease shows that the altered intermediate value affects continuation success.

Correctness before the receiver intervenes. We audited 2,400 prefixes from 100 difficulty-stratified MATH-500 problems, truncated at 25%, 50%, and 75% of the reasoning after removing the answer span. GPT-5.6-sol (high reasoning effort) and Claude Opus 5 judged whether the reasoning is correct throughout, without method identity or reference answer.

RLTR prefixes are more often correct: +4.2 pp [+1.0, +7.6] at 25% and +4.5 pp [+0.3, +9.0] at 50%, with 10,000 problem-level bootstrap resamples. The 75% difference is inconclusive (+2.8 pp [−1.7, +7.4]). The audit precedes the receiver, so receiver repair cannot explain it.

Successful continuation from naturally erroneous prefixes is uncommon. From the 293 audited prefixes that both judges flagged as erroneous, the 3B receiver reaches the correct answer in 7.8% of continuations. That is below its 26.7% accuracy on the same problems from the question alone, and below the original 7B model's 19.8%. The edited and natural-error sets are different populations, so their absolute rates should not be compared.

We agree that Maj@K and receiver utility alone do not establish logical correctness. The audit is our direct evidence on correctness, and the revision states our claims in these measured terms rather than as general robustness.

AuthorsOpenReview ↗

Response to Reviewer WhQ3 (2/3)

[W2 & Q1] Contribution relative to PAV and MRT; a progress reward with the same receiver

Our contribution is the reward construction, not the use of a second model. RLTR rewards the verified outcome of one fresh continuation, by a separate frozen receiver, from a randomly truncated prefix of the current generator. It needs neither a learned verifier nor differences between successive progress estimates.

PAV's RL experiments do not reward the policy through fresh prover continuations. Prover rollouts train a verifier, which then stays fixed and supplies step-level advantages [1]. MRT's open-ended implementation estimates progress with same-model best-guess probes after the thought block is terminated, together with continued-reasoning rollouts [2]. MRT's general formulation permits an external meta-prover, so what distinguishes RLTR is this construction, not the use of a second model.

To hold receiver choice fixed as you suggested, we ran our MRT-style progress baseline with the same frozen Qwen2.5-3B receiver. Entries are Acc. / Maj@64 (%).

Method / frozen continuation modelAIME2024AMC23MATH-500GSM8K
MRT-based / initial 7B13.7 / 17.853.4 / 63.377.0 / 83.091.7 / 94.2
MRT-based / 3B (new)13.8 / 16.753.7 / 60.076.8 / 83.091.8 / 94.0
RLTR-self / initial 7B11.1 / 16.753.6 / 62.577.0 / 82.891.7 / 93.4
RLTR / 3B14.8 / 21.153.5 / 67.577.0 / 84.292.0 / 94.2

With the receiver fixed at 3B, RLTR has higher Maj@64 on all four benchmarks: +4.4 on AIME2024, +7.5 on AMC23, +1.2 on MATH-500, and +0.2 on GSM8K, where both methods are near saturation (94%). Accuracy is higher on three benchmarks and 0.2 lower on AMC23. Moving the progress baseline to the 3B receiver does not reproduce RLTR's high-K performance.

Scope. Our baseline is the segment-wise GRPO adaptation in Appendix B.6, not an exact reproduction of MRT, and the comparison fixes receiver identity while varying the truncation boundaries, reward construction, and credit assignment together. It estimates progress at two randomly placed boundaries. At each one, the continuation model is stopped from reasoning further (the thought block is closed with </think>) and gives its best-guess answer four times, for eight short generations per response (243 generated tokens each on average). RLTR uses one full continuation of one random prefix (433 generated tokens on average). The baseline therefore generates about 4.5 times as many receiver tokens per response as RLTR (1,944 vs. 433), before counting its eight-fold input processing, so RLTR's advantage does not come from a larger continuation budget.

On the modest single-sample gains: we computed paired 95% intervals for six small-benchmark or small-gain settings. All six Maj@K intervals exclude zero, for example +3.1 pp [+1.0, +6.0] on AIME2025 with Qwen3-8B and +0.8 pp [+0.3, +1.5] on MathVista. The accuracy gains in those two settings and on AMC23 are positive but not individually conclusive (+0.5 pp [−1.7, +2.6], +0.3 pp [−0.4, +1.0], and +0.7 pp [−4.0, +4.9]); accuracy intervals exclude zero in the other three settings, and every point estimate favors RLTR.

References

[1] Amrith Setlur et al. Rewarding Progress: Scaling Automated Process Verifiers for LLM Reasoning. International Conference on Learning Representations, 2025.

[2] Yuxiao Qu et al. Optimizing Test-Time Compute via Meta Reinforcement Finetuning. International Conference on Machine Learning, 2025.

AuthorsOpenReview ↗

Response to Reviewer WhQ3 (3/3)

[Q3] How should the receiver be selected?

As a default, use the strongest available model that is still clearly weaker than the generator, from the same family when possible. All four of our settings follow this rule: Qwen2.5-3B for the Qwen2.5-7B generator, Qwen3-4B for Qwen3-8B, Llama-3.2-3B for Llama-3.1-8B, and Qwen2.5-VL-3B for Qwen2.5-VL-7B. Only the main setting includes a receiver ablation (Figure 4b).

Figure 4b supports both halves of this rule. A receiver as strong as the generator is not the best: the frozen initial 7B model gives lower Maj@16/64 than Qwen2.5-3B (82.3/82.8 vs. 83.8/84.2). Among weaker receivers, the stronger one is better at high K: Qwen2.5-3B is ahead of Qwen2.5-1.5B and Llama-3.2-3B at Maj@16/64, although Qwen2.5-1.5B has the best Maj@4 (79.6).

We expect this because the receiver must be weak enough that its success depends on the prefix, yet strong enough to finish a good one. The first half is visible in our audit: from erroneous prefixes, the original 7B model reaches the correct answer in 19.8% of continuations and the 3B receiver in 7.8%, so a stronger receiver more often rewards a flawed prefix.

This is a default that worked in the settings we tried, not a proven optimum. The comparison with Llama-3.2-3B does not isolate model family from capability, and we did not test receivers stronger than the generator. When several candidates qualify, held-out validation performance of the trained generator and training cost can break the tie.

On cost, the main setting gives a measured result: RLTR reaches 76.2% MATH-500 accuracy in 2.4 hours versus 4.8 for RLVR. The Qwen3 comparison is descriptive rather than a statistically established time-to-target improvement: the measured per-step cost ratio (1.53×) maps 60 RLTR steps to approximately 92 RLVR steps in time, and RLTR's validation mean at that point (65.6%) exceeds RLVR's highest mean over 150 steps (65.2%).


How your review improved the paper. Your suggestions led us to add controlled prefix edits that separate reasoning content from presentation (Appendix E.4) and a progress-reward control with the same receiver and its continuation budget (Appendix E.2), and to state our claims in measured terms rather than as general robustness.

We hope these additions address your concerns; if so, we would be grateful if you would consider updating your assessment.

Reviewer_jouFOpenReview ↗
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Paper summary

The paper proposes RLTR, which augments final-answer rewards with a reward for cross-model reasoning transfer. A trainable generator produces a solution, and a frozen receiver continues from a randomly truncated reasoning prefix. The receiver’s final-answer correctness provides an additional reward for training the generator. Experiments report improvements in average accuracy and majority-vote performance over RLVR, along with faster convergence. Further analyses examine different receivers, truncation strategies, and the usefulness of generated prefixes for models not used during training.

Critical strengths
  1. The paper introduces a simple auxiliary reward based on whether another model can successfully continue a reasoning prefix. This provides verifiable feedback without training a separate reward model.

  2. The experiments cover mathematical, scientific, coding, and visual reasoning tasks. Ablations examine reward weights, receiver choice, and truncation strategies, while comparisons with self-continuation help assess the value of using a separate receiver.

  3. The paper evaluates prefix utility for receivers not used during training and reports both training compute and wall-clock costs. These analyses go beyond final accuracy to examine transferability and practical efficiency.

Critical weaknesses
  1. The receiver may reach the correct answer by fixing mistakes in the prefix. This makes it difficult to determine whether RLTR improves the reliability of the generator’s reasoning or produces prefixes that the receiver can more easily work with. Further analysis of how receivers use and revise the supplied prefixes would help clarify the source of the improvement.

  2. Some gains are modest, including 0.5 points on AIME2025 with Qwen3-8B and 0.3 points on MathVista. Paired confidence intervals would clarify whether these improvements are reliable, especially on small benchmarks.

  3. The training-efficiency analysis focuses on the main MATH-500 setting. It remains unclear whether the compute and wall-clock advantages persist with larger training datasets, stronger generators, or different receivers.

Questions for authors
  1. Does RLTR reduce intermediate reasoning errors, beyond improving receiver success? An evaluation of step-level correctness would help clarify what changes in the generated reasoning.

  2. Could you report paired confidence intervals for the improvements over RLVR, particularly on the smaller competition benchmarks and settings with modest gains?

  3. Do the training-efficiency gains persist with stronger generators or larger training datasets? Accuracy-versus-compute curves beyond the main MATH-500 setting would help assess this.

2 comments
AuthorsOpenReview ↗

Response to Reviewer jouF (1/2)

Thank you for the constructive review. We added the correctness audit, the paired intervals, and the stronger-generator curves you asked for.


[W1 & Q1] Does RLTR reduce intermediate reasoning errors, or does the receiver repair the prefix?

RLTR improves judged prefix correctness before receiver intervention, so these correctness gains cannot be attributed to receiver-side repair. The generator's own accuracy and Maj@K improve with no receiver at test time, and a receiver never used in training benefits at short prefixes (Table 9). Nevertheless, neither result measures step-level correctness, so we ran the audit you asked for.

We sampled 100 MATH-500 problems (20 per difficulty level) and four solutions per method and problem. After removing the terminal answer span, each solution was truncated at 25%, 50%, and 75% of its reasoning length, giving 2,400 prefixes. GPT-5.6-sol (high reasoning effort) and Claude Opus 5 independently judged whether all mathematical reasoning in a prefix is correct, seeing only the problem and the prefix. Scores are averaged over the two judges; 95% CIs use 10,000 problem-level bootstrap resamples.

Prefixes judged correct throughout (%)25%50%75%
RLVR88.180.178.3
RLTR92.484.681.1
RLTR − RLVR, pp [95% CI]+4.2 [+1.0, +7.6]+4.5 [+0.3, +9.0]+2.8 [−1.7, +7.4]

RLTR prefixes are more often correct at 25% and 50% of the reasoning, with intervals excluding zero. The 75% difference is positive but inconclusive. Because the audit precedes the receiver, receiver-side correction cannot explain these differences.

Successful continuation from naturally erroneous prefixes is uncommon for the receiver. We took the 293 audited prefixes that both judges flagged as erroneous and sampled three continuations per prefix from each model.

Evaluation conditionAccuracy (%)
Original Qwen2.5-7B, erroneous prefix19.8
Receiver Qwen2.5-3B, erroneous prefix7.8
Receiver Qwen2.5-3B, question only (no prefix)26.7

The 3B receiver reaches the correct answer in 7.8% of these continuations, compared with 26.7% on the same problems from the question alone. Its success rate is also lower than the original 7B model's (7B − 3B: +12.0 pp [+7.2, +16.7]). These numbers do not show whether a success is a repair or a fresh solution; repair may still occur, and a positive transfer reward does not certify an error-free prefix.

Together with the controlled-edit results, this supports the interpretation that the transfer reward is sensitive to errors in intermediate reasoning.

Which response receives the reward also matters: permuting transfer rewards within a group (RLTR-shuffled, Table 11) preserves the group's transfer-reward values but does not recover RLTR's Maj@16 or Maj@64 on any benchmark.


[W2 & Q2] Are the modest gains reliable?

Yes for Maj@K in all six reported settings: all six intervals exclude zero, covering the small competition benchmarks and the modest gains you highlighted. For accuracy, three of six intervals exclude zero and every point estimate favors RLTR.

Paired 95% confidence intervals for RLTR − RLVR, in percentage points. With the problem set held fixed, each bootstrap replicate resamples the three training seeds with replacement and, within each selected seed, the generations for each problem (up to 64 per seed); the protocol is in Appendix E.3.

Generator / benchmarkΔ Acc.95% CIΔ Maj@K95% CI
Qwen2.5-7B / AIME2024+3.2[+1.1, +5.9]+2.2 (K=64)[+0.3, +3.9]
Qwen2.5-7B / AMC23+0.7[−4.0, +4.9]+5.8 (K=64)[+1.5, +10.5]
Qwen3-8B / AIME2024+1.2[+0.1, +1.9]+4.4 (K=32)[+0.2, +8.9]
Qwen3-8B / AIME2025+0.5[−1.7, +2.6]+3.1 (K=32)[+1.0, +6.0]
Qwen2.5-VL-7B / MMK12+1.4[+0.9, +1.9]+3.2 (K=16)[+2.1, +4.4]
Qwen2.5-VL-7B / MathVista+0.3[−0.4, +1.0]+0.8 (K=16)[+0.3, +1.5]

Accuracy intervals exclude zero for both AIME2024 configurations and for MMK12. The accuracy differences on AMC23 (+0.7), AIME2025 (+0.5), and MathVista (+0.3) are positive but not individually conclusive, while the Maj@K gains in the same three settings exclude zero (+5.8, +3.1, and +0.8).

AuthorsOpenReview ↗

Response to Reviewer jouF (2/2)

[W3 & Q3] Do the efficiency gains persist with a stronger generator or a larger training set?

The Qwen3 results provide additional evidence of an efficiency benefit after accounting for the measured per-step overhead. With a Qwen3-8B generator trained on Polaris and a frozen Qwen3-4B receiver, RLTR keeps an advantage after accounting for its measured per-step overhead.

At the same step, RLTR has the higher mean validation accuracy at 14 of the 15 evaluation points (every 10 steps from 10 to 150). Means and standard deviations are over three training runs per method.

Polaris validation accuracy, mean ± SD (%)RLVRRLTRDifference, pp
Step 6062.4 ± 0.965.6 ± 2.0+3.2
Step 12064.2 ± 2.068.6 ± 1.6+4.4
Step 15063.6 ± 1.565.6 ± 2.0+2.0

RLTR's per-step wall-clock cost in this setting is about 1.53× that of RLVR (the ratio of mean training-step durations), so 60 RLTR steps correspond to approximately 92 RLVR steps in time. At that point RLTR's mean (65.6%) exceeds the highest RLVR mean at any evaluation point up to step 150 (65.2%). This is a comparison of recorded means, not a statistically established time-to-target improvement. Figure 8 shows the full learning curves by training step, and Appendix E.6 specifies the timing calculation.

The overhead is larger than in the main setting (1.25×). Qwen3-8B is run with a 16,384-token maximum generation length (8,192 in the main setting) and typically produces much longer reasoning, which may contribute to the difference. Part of the overhead is implementation cost: the receiver is loaded and unloaded in verl at each step. That part could be reduced with further engineering; we report the unoptimized figure.

We do not claim a universal speedup factor. In the main setting, the improvement is measured directly: RLTR reaches 76.2% MATH-500 accuracy in 40 steps and 2.4 hours, versus 100 steps and 4.8 hours for RLVR, including receiver computation and averaged over three runs per method.


How your review improved the paper. Your questions led us to add a blinded audit of prefix correctness with a natural-error diagnostic (Appendix E.1), paired confidence intervals for the small-benchmark and small-gain settings (Appendix E.3), and Qwen3 learning curves with the per-step cost accounted for (Appendix E.6).

We hope these additions address your concerns; if so, we would be grateful if you would consider updating your assessment.

Comments on the paper

1 comment
AuthorsOpenReview ↗

General Response

We thank the reviewers for their careful and constructive assessments. All three found RLTR simple to add to an existing RL pipeline, with a directly verifiable auxiliary reward that needs no separately trained reward model. They also recognized the breadth of the evaluation across backbones and across mathematical, scientific, coding, and visual reasoning (jouF, WhQ3), the controls for alternative explanations (8b7n), and efficiency evidence that includes receiver cost and wall-clock time. The concerns centered on mechanism, attribution, statistical reliability, and compute accounting. We summarize below how each was addressed; every individual response is self-contained.

How we addressed the concerns

  1. Does RLTR improve the reasoning itself? (jouF W1, WhQ3 W1, 8b7n W2) A blinded audit of 2,400 prefixes finds higher correctness before receiver continuation: +4.2 pp [+1.0, +7.6] at 25% and +4.5 pp [+0.3, +9.0] at 50%. Controlled edits show sensitivity to injected mathematical errors (−10.44 pp), with little change under the tested prose rewrites (−0.18 pp).
  2. Receiver choice or reward construction? (WhQ3 W2, 8b7n W1) With the same frozen 3B receiver, RLTR retains higher Maj@64 than the MRT-style progress baseline on all four benchmarks. The baseline generates about 4.5 times as many receiver tokens per response, so the gain does not come from a larger continuation budget. We clarify the reward-construction distinction from PAV/MRT and the remaining differences in truncation and credit assignment.
  3. Are longer prefixes responsible? (8b7n W2) At fixed budgets of 128, 256, and 384 tokens, all six point estimates favor RLTR. Three intervals exclude zero, including the held-out receiver at 128 tokens with 100% coverage.
  4. Are modest gains reliable? (jouF W2, WhQ3 W2) The AMC23, AIME2025, and MathVista accuracy gains remain inconclusive, but paired 95% intervals exclude zero for Maj@K in all six reported settings and for accuracy in three.
  5. Does efficiency extend beyond the main setting? (jouF W3, WhQ3 Q3, 8b7n Q3) With Qwen3-8B, RLTR's mean validation accuracy keeps an advantage over RLVR's after converting steps to time with the measured 1.53× per-step cost. Only the main setting's speedup is a directly measured wall-clock time; the FLOPs figures are analytical estimates under fixed lengths.
  6. How should the receiver be chosen? (WhQ3 Q3) As a default, the strongest available model that is still clearly weaker than the generator, which is the rule we followed in all four generator settings. A receiver as strong as the generator is not better in our ablation.

Where to find the changes in the revision

Changes are marked in blue.

  • Main text. The introduction scopes the contribution to the reward construction and scopes prefix-utility claims by receiver and interruption point. Section 3.1 states robustness in measured terms. Section 3.3 reports the same-receiver result and describes RLTR-self as a frozen copy of the initial generator. Section 3.4 summarizes the correctness audit, the controlled edits, and the fixed-length control, and labels the 7.2% FLOPs overhead as an analytical estimate under fixed-length assumptions.
  • Appendix E (new). E.1: correctness and natural-error audits (Tables 15–16). E.2: same-receiver comparison (Table 17). E.3: paired intervals and the resampling protocol (Table 18). E.4: controlled edits (Table 19). E.5: length statistics with fixed-length and correctness-stratified controls (Tables 20–22). E.6: Qwen3 learning curves with the timing calculation specified (Table 23, Figure 8).
  • Appendix B.2. FLOPs assumptions, the length-sensitivity calculation, and measured wall-clock time.
  • AI Use Statement. Covers the LLM-judged audit and the LLM-generated presentation edits.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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