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Paper summary
This paper proposes Reinforcement Learning with Transferable Reward (RLTR), which augments outcome-based reinforcement learning with feedback from another model’s continuation of a reasoning prefix. The generator first produces a complete solution. A randomly retained fraction of its reasoning, excluding the terminal answer span, is then supplied to a frozen receiver. The correctness of one sampled receiver continuation provides an auxiliary reward, which is combined with the generator’s answer and format rewards to train the generator using GRPO. The method does not require training a separate process reward model. The principal evaluation uses a Qwen2.5-7B-Instruct generator and a Qwen2.5-3B-Instruct receiver, with additional experiments on stronger language models, another model family, and vision-language reasoning. The paper reports improvements in average accuracy and majority-vote accuracy, reduced training cost to reach a target accuracy, and improved prefix utility for held-out receivers. It also compares against process-reward, frozen self-continuation, and MRT-style progress baselines.
Critical strengths
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A simple training modification produces practically relevant performance and efficiency gains. RLTR adds a directly verifiable auxiliary signal without requiring a separately trained process reward model. The reported improvements are not restricted to the receiver-continuation metric being optimized: the generator itself improves. For example, Table 11 reports MATH-500 average accuracy increasing from 76.2 to 77.0 and Maj@64 from 82.2 to 84.2 relative to RLVR; AMC23 Maj@64 increases from 61.7 to 67.5. The Qwen3 and Llama experiments provide additional evidence that the effect is not specific to the main generator checkpoint. These results make the method potentially useful as a relatively simple addition to an existing RL training pipeline.
Importantly, the efficiency evidence goes beyond counting optimization steps. Table 2 reports reaching 76.2% MATH-500 accuracy in 2.4 hours with RLTR versus 4.8 hours with RLVR, while explicitly including the additional receiver computation in the comparison. This is a consequential practical result, although the precise FLOP accounting would benefit from the clarification requested below. -
The paper includes meaningful controls for several obvious alternative explanations. The experimental design is substantially stronger than a comparison against outcome-only RL alone. Appendix A.3 specifies three training seeds and checkpoint selection on a separate validation set, without using test performance for selection. Appendix B.6 includes both frozen self-continuation and a progress-based control, as well as a reward-assignment control that permutes transfer rewards among responses to the same problem. The latter is especially useful because it tests whether assigning receiver feedback to the particular response that produced it matters, rather than merely reproducing the within-group distribution of auxiliary rewards.
The held-out receiver evaluation also includes question-only, shuffled-prefix, and answer-masked conditions. In Table 9, the masked RLTR–RLVR differences remain positive with confidence intervals excluding zero at truncation ratios 0.3 and 0.5. This provides evidence that the observed advantage is not explained solely by the explicit answer spans removed by the masking procedure. These controls materially strengthen the empirical case for useful prefix-dependent supervision.
Critical weaknesses
- The distinctive contribution and the attribution to “cross-model transfer” remain only partly isolated. In expectation, the transfer reward estimates a frozen receiver’s probability of successful continuation from a prefix. The broader idea of improving a policy using another, potentially weaker, prover’s assessment of intermediate progress already appears in Rewarding Progress / PAV. That work explicitly emphasizes complementary prover policies distinct from the base policy. RLTR’s meaningful distinction is therefore its direct online continuation feedback, random-prefix construction, and avoidance of a learned process verifier—not the use of another model’s reasoning ability by itself. The submission acknowledges this related work, but the conceptual contribution should remain scoped accordingly. The receiver comparisons do not fully resolve this distinction. RLTR-self uses a frozen copy of the initial 7B generator, rather than the current policy, while the main method uses a separately pretrained 3B receiver. This changes receiver capacity and continuation behavior as well as its relationship to the generator. The MRT-based control also uses the frozen initial-policy prover and changes the reward construction and credit assignment. Consequently, Table 11 demonstrates that the selected RLTR configuration performs well, but does not cleanly establish whether the decisive factor is cross-model transfer, a better-calibrated receiver, or the particular auxiliary-reward construction. A progress-based comparison using the same 3B receiver would be especially informative. This limits the strength of the claimed mechanistic contribution, although it does not negate the practical results.
- Relative-length truncation leaves an important token-budget confound in the interpretation of prefix utility. The retained prefix length is defined as a fraction of the generator’s completed reasoning length. Thus, the same truncation ratio does not necessarily expose the receiver to the same number of tokens across methods. Longer generated solutions could supply longer prefixes at every ratio, potentially improving continuation accuracy without improving the usefulness of reasoning at a fixed token budget. Because the boundary depends on the completed trace length, this is relevant to both the evaluation and the incentives induced during training. The manuscript does not report the corresponding trace-length distributions or fixed-absolute-prefix-length comparisons. This is a possible alternative explanation, not evidence that the model actually exploits it.
The existing masking and shuffled-prefix controls are valuable, but address different questions. Moreover, the held-out gains are not uniformly decisive: for the Llama receiver, the genuine-prefix differences at ratios 0.5 and 0.7 are +0.73 and +0.27 percentage points, with both confidence intervals including zero. The evidence therefore supports useful transfer in some conditions more strongly than a general improvement across interruption points. Reporting fixed-token comparisons, together with actual generator and receiver token counts, would substantially strengthen the reasoning-quality interpretation and help validate the precise computational-overhead estimates. Table 8 currently assigns identical generator-side FLOPs to the two methods, making the assumptions behind this accounting particularly relevant.
Questions for authors
- Please report the generator reasoning-length and retained-prefix-length distributions for RLVR and RLTR. Can the held-out continuation comparison be repeated at fixed absolute prefix lengths, with matched receiver continuation budgets? This would help distinguish improved prefix usefulness from providing the receiver with more generated context. A correctness-stratified comparison would additionally help separate prefix quality from differences in the frequency of successful generator solutions.
- The self-continuation and MRT-based controls use the frozen initial 7B policy, whereas RLTR uses the 3B receiver. How does an MRT-style progress reward perform when estimated using the same frozen 3B receiver under a comparable continuation budget? Such a comparison would materially affect my assessment of whether the contribution is principally the receiver choice or the transfer-reward construction. Please also distinguish conclusions about frozen initial-policy continuation from conclusions about continuation by the current policy.
- Are the FLOPs in Tables 2 and 8 computed from actual executed sequence lengths, padded lengths, or configured maximum lengths? Does the receiver rollout cost include processing the question and transferred prefix as well as generating the continuation? Please explain the identical generator-side costs in Table 8 and clarify whether the wall-clock measurements use identical hardware allocations and include all method-specific training operations. The wall-clock result is already useful; these details would determine how strongly I interpret the reported approximately 7% FLOP overhead and its likely generality.
5 comments
Response to Reviewer 8b7n (2/3)
[W2 & Q1] Is prefix utility explained by longer prefixes under relative-length truncation?
Longer prefixes alone do not explain the observed advantage: gains remain in several fixed-token conditions, including a held-out receiver at 100% coverage. At fixed absolute prefix lengths, every point estimate still favors RLTR, for both the training receiver and a held-out one. Nevertheless, your concern is well founded, because RLTR's solutions are longer on average. We therefore tested it directly, as you suggested.
Length statistics (MATH-500 evaluation outputs, Qwen2.5 tokens).
| Token-length statistic | RLVR | RLTR |
|---|---|---|
| Mean generation length | 600 | 694 |
| Median generation length [P25, P75] | 485 [343, 752] | 481 [343, 786] |
| Mean retained prefix length at 30% / 50% / 70% | 180 / 300 / 419 | 208 / 347 / 485 |
RLTR's mean length is 15.7% higher while the medians are similar.
Fixed prefix budgets. Each row uses the solution pairs eligible under both methods. Within each receiver, both methods share the same continuation cap, a maximum of 8,192 generated tokens. Prefix budgets are counted with the Qwen2.5 tokenizer for both receivers.
| Receiver | Prefix tokens | Eligible n (coverage) | RLVR (%) | RLTR (%) | RLTR − RLVR, pp [95% CI] |
|---|---|---|---|---|---|
| Qwen2.5-3B (training) | 128 | 2,000 (100%) | 60.3 | 61.0 | +0.72 [−0.53, +2.00] |
| Qwen2.5-3B (training) | 256 | 1,787 (89.3%) | 59.4 | 61.3 | +1.90 [+0.40, +3.43] |
| Qwen2.5-3B (training) | 384 | 1,213 (60.6%) | 50.3 | 53.1 | +2.86 [+0.91, +4.78] |
| Llama-3.1-8B (held-out) | 128 | 2,000 (100%) | 33.3 | 35.1 | +1.80 [+0.38, +3.20] |
| Llama-3.1-8B (held-out) | 256 | 1,787 (89.3%) | 35.0 | 36.4 | +1.46 [−0.28, +3.21] |
| Llama-3.1-8B (held-out) | 384 | 1,213 (60.6%) | 29.8 | 30.8 | +0.93 [−0.89, +2.76] |
Intervals exclude zero for the training receiver at 256 and 384 tokens, and for the held-out receiver at 128 tokens, where coverage is 100%. The other three differences are positive but inconclusive, and we do not claim a gain in every condition. Eligibility changes with the budget, so comparisons are valid within rows, not across them.
Correctness-stratified comparison (training receiver, 256 tokens, same-problem solution pairs).
| Original generator outcomes | RLVR receiver acc. (%) | RLTR receiver acc. (%) | Difference, pp [95% CI] |
|---|---|---|---|
| Both correct | 78.3 | 80.1 | +1.73 [+0.11, +3.34] |
| Both incorrect | 7.4 | 8.8 | +1.47 [−0.64, +3.70] |
Among pairs where both generators are correct, RLTR prefixes still help more. A higher rate of correct full solutions therefore cannot by itself explain the advantage within this subset. The both-incorrect difference is positive but inconclusive.
Separately, a blinded audit finds RLTR prefixes more often correct before any receiver continuation. On 2,400 prefixes from 100 MATH-500 problems, two LLM judges saw only the problem and the prefix. The difference is +4.2 pp [+1.0, +7.6] at 25% of the reasoning and +4.5 pp [+0.3, +9.0] at 50%; at 75% it is inconclusive (+2.8 pp [−1.7, +7.4]).
The revision states that prefix-utility gains depend on the receiver and the interruption point, rather than describing them as uniform.
Response to Reviewer 8b7n (3/3)
[Q3] How were FLOPs and wall-clock time computed?
The FLOPs in Tables 2 and 8 are analytical estimates at the configured maximum generation length (8,192 tokens), not executed or padded lengths. Both methods were assigned a 512-token prompt and this 8,192-token maximum, which is why the generator-side entries are identical. The receiver entry (66.49 PFLOPs) uses the same assumption and includes input processing.
Length sensitivity. Substituting the MATH-500 evaluation mean generation lengths (600 vs. 694 tokens) gives generator-side costs of 99.45 vs. 108.11 PFLOPs per step, an 8.7% increase. This sensitivity calculation uses different length assumptions from the 7.2% receiver-overhead estimate in Table 8, so the two estimates should be interpreted separately. The measured per-step wall-clock overhead is 25.2%, including receiver loading and unloading in verl and all other method-specific operations.
Executed lengths. The receiver's continuations averaged 433 generated tokens per response in training, far below the configured maximum. Run-wide FLOPs accounting would also require the generator's executed lengths during training and the corresponding padding and batching conventions.
Wall-clock. Our efficiency claim rests on measured time to the same accuracy: 76.2% on MATH-500 after 40 steps and 2.4 hours for RLTR, versus 100 steps and 4.8 hours for RLVR. All runs used the same hardware allocation, and the measurement includes every RLTR-specific operation, including loading and unloading the receiver in verl at each step.
Part of the per-step overhead (1.25× in the main setting, 1.53× with Qwen3) therefore reflects our implementation rather than receiver computation, and could be reduced with further engineering. We report the unoptimized figure. The revision separates analytical estimates, the length-sensitivity calculation, and measured wall-clock time.
How your review improved the paper. Your review led us to add the same-receiver progress control with its continuation budget (Section 3.3, Appendix E.2), fixed-prefix-length and correctness-stratified evaluations with length statistics (Appendix E.5), and a corrected account of our compute estimates (Appendix B.2), and to scope the contribution statement in your terms.
We hope the result and these additions address your concerns; if so, we would be grateful if you would consider updating your assessment.
Response to Reviewer 8b7n (1/3)
Thank you for the detailed assessment. We added the same-receiver progress control, fixed-prefix-length and correctness-stratified evaluations, and a corrected account of our compute estimates.
[W1 & Q2] Receiver choice or transfer-reward construction? Relation to PAV and MRT
The same-receiver control shows that receiver identity alone does not explain the advantage of the evaluated RLTR configuration.
The generator is rewarded with the checked outcome of one fresh continuation, by a separate frozen receiver, from a randomly truncated prefix of its current reasoning. This adds a process-level signal to RLVR at the cost of one extra rollout: no learned process verifier is trained or queried, and no step segmentation or progress differences are computed. It improves the generator's own accuracy and Maj@K, keeps Pass@64 close to the base model's level where RLVR lowers it (95.0 vs. 92.2 on MATH-500), and halves the wall-clock time to RLVR's accuracy (2.4 vs. 4.8 hours).
Relation to PAV and MRT. As you note, using a second model is not what is new. In your words, RLTR's distinction is its "direct online continuation feedback, random-prefix construction, and avoidance of a learned process verifier," and the revised contribution statement adopts this scope. PAV's RL pipeline rewards the policy through a fixed verifier trained on prover rollouts, not through fresh prover continuations [1]. MRT's open-ended implementation combines same-model thought-termination probes with continued reasoning to estimate progress [2], and its general formulation permits an external meta-prover. RLTR instead rewards one receiver continuation of a random prefix directly.
Receiver choice versus reward construction. We ran our MRT-style progress baseline with the same frozen Qwen2.5-3B receiver, as you suggested. Entries are Acc. / Maj@64 (%).
With the receiver fixed at 3B, RLTR has higher Maj@64 on all four benchmarks: +4.4 on AIME2024, +7.5 on AMC23, +1.2 on MATH-500, and +0.2 on GSM8K, where both methods are near saturation (94%). Accuracy is higher on three benchmarks and 0.2 lower on AMC23. We read this as an advantage for the evaluated RLTR configuration, not universal superiority of transfer over progress rewards; within that scope, moving the progress baseline to the 3B receiver does not reproduce RLTR's high-K performance.
Frozen initial policy versus current policy. Both 7B controls (RLTR-self and MRT-based / 7B) continue from a frozen copy of the initial generator, not from the updated policy. We draw no conclusion about continuation by the current policy, and Section 3.3 now makes this explicit.
Budget. The MRT-style control keeps Appendix B.6's segment-wise construction with two randomly placed boundaries, and the comparison fixes receiver identity while varying the truncation boundaries, reward construction, and credit assignment together. At each boundary, the continuation model is stopped from reasoning further (the thought block is closed with
</think>) and gives its best-guess answer four times, for eight short generations per response (243 generated tokens each on average). RLTR uses one full continuation of one random prefix (433 generated tokens on average). The control therefore generates about 4.5 times as many receiver tokens per response as RLTR (1,944 vs. 433), before counting its eight-fold input processing, so RLTR's advantage does not come from a larger continuation budget.References
[1] Amrith Setlur et al. Rewarding Progress: Scaling Automated Process Verifiers for LLM Reasoning. International Conference on Learning Representations, 2025.
[2] Yuxiao Qu et al. Optimizing Test-Time Compute via Meta Reinforcement Finetuning. International Conference on Machine Learning, 2025.