acceptodds
Under review as a conference paper at ICLR 2027

RLVR Training of LLMs Does Not Improve Thinking Ability for General QA: Evaluation Method and a Simple Solution

Abstract

Reinforcement learning from verifiable rewards (RLVR) stimulates the thinking processes of large language models (LLMs), substantially enhancing their reasoning abilities on verifiable tasks. It is naturally assumed that similar gains should transfer to general question answering (GQA), but this assumption has not been thoroughly validated. To assess whether RLVR effectively improves LLM performance on GQA, we propose a Cross-Generation evaluation framework that measures the quality of intermediate thinking by feeding the generated thinking context into LLMs of varying capabilities. Our evaluation leads to a discouraging finding: the efficacy of the thinking process on GQA tasks is markedly lower than on verifiable tasks, suggesting that explicit training on GQA remains necessary in addition to training on verifiable tasks. We further observe that direct RL training on GQA is less effective than RLVR. Our hypothesis is that, whereas verifiable tasks demand robust logical chains to obtain high rewards, GQA tasks often admit shortcuts to high rewards without cultivating high-quality thinking. To avoid possible shortcuts, we introduce a simple method, Separated Thinking And Response Training (START), which first trains only the thinking process, using rewards defined on the final answer. We show that START improves both the quality of thinking and the final answer across several GQA benchmarks and RL algorithms.

Primary area:
reinforcement learning
Keywords:
Reinforcement Learning, Post training, Large Language Model

Reviews

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1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_6NdPOpenReview ↗
Rating
1
Confidence
3
Informativeness
1
Presentation
2
Soundness
1
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Paper summary

This paper examines whether reasoning skills from RLVR training in math and coding transfer to GQA. The authors find a significant gap: thinking traces help with formal tasks like MATH, but provide little benefit for GQA. To address this, they propose START, a two-stage approach that masks answers during training to force better thinking in phase 1, then optimizes thinking and answering together in phase 2. Experiments show START eliminates thinking stagnation and outperforms standard joint RL training.

Critical strengths

S1. START enables robust thinking evolution through a simple token-level gradient mask during backpropagation. It works well with existing open-source RL frameworks like GRPO and DAPO.

Critical weaknesses

W1. The title claims findings about RLVR, but the GQA experiments use learned reward models (ArmoRM), not verifiable rewards. The MATH comparison changes both task domain and reward mechanism simultaneously, making it unclear which causes the observed thinking stagnation. Please clarify this distinction and limit claims to what the experiments actually demonstrate.

W2. Masking answer-token gradients does not freeze answering behavior. Because thinking and answering share model parameters, updates from thinking tokens still affect the answer distribution. Table 5 confirms this: answering improves by +0.0055 during Phase I, surpassing the +0.0046 gain from updated thinking alone. This contradicts START's central claim that answering becomes stationary and that rewards improve solely through better thinking.

Questions for authors

Q1.How sensitive is START’s performance to the transition point between Phase 1 and 2? Could the authors provide an ablation varying Phase 1 duration under a fixed total training budget, and guidance on selecting the transition point for new model families or task distributions?

6 comments

We sincerely thank you for your careful review and valuable comments. Below, we provide point-by-point responses to each comment.

W1: Regarding GQA with Learned Reward Models

R: We thank the reviewer for highlighting this distinction. RLVR applies to tasks such as MATH, where correctness can be deterministically verified. When transferring to open-ended GQA, such verifiable rewards are no longer available. We therefore use ArmoRM, a multi-objective reward model that evaluates response quality across multiple preference dimensions (correctness, truthfulness, instruction following), to provide comprehensive feedback for open-ended answers. Thus, the change in reward type follows inherently from the change in task domain, rather than representing an independently varied experimental factor.

To directly evaluate the title claim, we further tested the Qwen3-1.7B model trained on MATH with GRPO on ExpertQA. Its post-RLVR thinking traces, paired with the base answerer, achieve a 45.54% win rate against the base configuration, while the full post-trained model achieves 49.17%. These results provide direct evidence that, in this setting, the thinking improvements obtained through RLVR do not transfer to GQA. We have clarified the distinction between verifiable rewards and learned rewards in the revision.

ConfigurationRewardWin Rate (vs. Base)
Qwen3-1.7B0.1842-
Tpost+ApreT_{post} + A_{pre}0.183745.54%
Tpre+ApostT_{pre} + A_{post}0.184451.59%
Post-trained0.184049.17%

W2: Regarding Answering Behavior during Phase I

R: We thank the reviewer for identifying this overstatement. Masking answer tokens removes their direct contribution to the policy-gradient objective, but shared-parameter updates still change the answer distribution. The +0.0055+0.0055 gain for Tpre+ApostT_{pre}+A_{post} shows that Phase I improves both answering behavior and thinking utility; the reward gain should not be attributed solely to thinking. We have therefore replaced “fixed,” “stationary,” and “solely” with the more precise claim that Phase I focuses direct optimization on thinking tokens. Importantly, Tpost+ApreT_{post}+A_{pre} still achieves a +0.0046+0.0046 gain and a 69.11% win rate when evaluated with the unchanged base answerer, demonstrating improved functional utility of the learned thinking traces.

Q1: Regarding Phase Transition Sensitivity

R: START does not use a predetermined transition step. Phase II begins when the validation Tpost+ApreT_{post}+A_{pre} reward shows no improvement for three consecutive evaluations (approximately 600 steps in our main setting). We also forced an earlier transition at 300 steps while keeping the total training budget fixed:

ModelPost-trained RewardPost-trained Win RateTpost+ApreT_{post}+A_{pre} RewardTpost+ApreT_{post}+A_{pre} Win Rate
GRPO0.2182—0.1849—
+START (300-step Phase I)0.219158.92%0.185552.55%
+START0.220159.24%0.187668.15%

The early transition mainly weakens standalone thinking utility (52.55% vs. 68.15%). For new models or datasets, we recommend monitoring Tpost+ApreT_{post}+A_{pre} on the validation set and transitioning after three evaluations without improvement. We have added this ablation to the revision.

Thanks for the detailed explanation. RLVR is inherently designed for verifiable tasks, whereas adapting it to GQA relies on a model-based scorer. This raises two lingering questions:

  1. Comparison with non-RL baselines: RLVR has gained popularity for its effectiveness in enhancing LLM reasoning and achieving superior performance over non-RL methods like SFT. Without comparing against non-RL baselines on GQA, it remains unverified whether explicit RL-based post-training is necessary for general QA tasks.

  2. Reward hacking and upper bound: Unlike verifiers in mathematics, a learned reward model is inherently subjective and susceptible to reward hacking. Also, does the quality of the reward model act as an upper bound on START's performance? If so, why don't we just use the reward model instead?

Q1: Comparison with Non-RL Baselines

R: We thank the reviewer and would like to clarify the scope of our claim.

We do not claim that RL post-training is necessary for GQA final performance, nor that it outperforms SFT. Our claim is: (i) in Section 2.1, we show that GQA thinking efficacy is low and not saturated (ii) our goal is to improve thinking itself; (iii) improving thinking typically requires RL, because SFT and distillation can only imitate an existing answer or thinking distribution, and open-ended GQA provides no gold thinking traces.

A non-RL baseline would test a different question, namely whether SFT can reach a similar final GQA score, and would require oracle supervision unavailable in most open-ended GQA settings. We therefore do not include it.

Q2: Reward Hacking and the Upper Bound of the Reward Model

R:

Reward hacking. We agree that using ArmoRM for both training and evaluation cannot by itself exclude reward over-optimization. We therefore re-evaluated the main comparisons with the independent Llama3-70B judge.

For Table 3, the win rates against the post-trained GRPO baseline are:

Config.Post-trainedTpost+ApreT_{post} + A_{pre}
GRPO------
GRPO-MA45.22%49.68%
+START52.23%59.23%

For Table 4, START's win rates against the respective vanilla post-trained baselines are:

SettingSTART Win Rate
ExpertQA / Qwen3-1.7B / DAPO56.41%
UltraFeedback / Qwen3-1.7B / GRPO53.75%
AlpacaEval / Qwen3-1.7B / GRPO52.05%
ExpertQA / Hunyuan-1.8B / GRPO56.05%
ExpertQA / Qwen3-4B / GRPO54.14%

The independent-judge margins are smaller than the ArmoRM-based ones (e.g., 59.23% vs. 68.15% for Tpost+ApreT_{post}+A_{pre}), but START remains above 50% in all five settings and the ranking is preserved.

Upper bound. We agree that the fidelity of the reward model bounds how faithful the training signal is, which is a general limitation of learned-reward RL. This bounds signal quality, not the answer quality the policy can reach: the RM is a scoring function rather than a generator, and its preferences define an ordering over responses rather than a ceiling on achievable quality. START is reward-agnostic in this sense—it changes how a given signal is allocated between thinking and answering. Therefore we cannot "just use the reward model instead": scoring answers is not producing them.

Reviewer_qJeROpenReview ↗
Rating
2
Confidence
3(+1)
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper studies whether thinking abilities learned through RLVR transfer to general question answering (GQA). The authors introduce Cross-Generation evaluation to separate the contributions of thinking and answering. They observe “thinking stagnation”: standard RL improves answering but does little to improve the usefulness of thinking traces. To address this, they propose START, a two-stage method that first masks gradients on answer tokens to focus training on thinking, then jointly trains thinking and answering. Across several GQA benchmarks and RL algorithms, START improves both final answer quality and the measured usefulness of thinking traces over standard RL.

Critical strengths
  1. The paper addresses an important question: whether the benefits of RLVR extend to thinking in general QA. Cross-Generation evaluation offers a useful way to examine how thinking and answering each contribute to performance.
  2. START is simple and requires only minor changes to existing RL training pipelines. The consistent gains across multiple GQA datasets, model architectures, and RL algorithms make the approach practically appealing.
Critical weaknesses
  1. The claim that RLVR does not improve thinking on general QA tasks is not fully supported by the experiments. A direct comparison of GQA thinking quality before and after RLVR training on verifiable tasks is missing. The Cross-Generation results show differences in the usefulness of thinking traces, but these alone do not establish a lack of transfer. 2.The rationale for Phase I needs clarification. The authors describe answer generation as a fixed part of the environment when gradients on answer tokens are masked. However, thinking and answering share model parameters, so this masking does not guarantee that the answering policy stays fixed. Table 5 also shows substantial improvements in answering during Phase I, which are difficult to reconcile with this explanation.
Questions for authors
  1. Could the authors directly compare GQA thinking quality before and after RLVR training on verifiable tasks to support the central claim?
  2. Given the shared parameters, what keeps the answering policy fixed during Phase I? How do the authors explain the answering gains in Table 5?
  3. Could the authors include ablations with thinking-only training and a truly frozen answering policy, using matched computational budgets?
  4. Could the authors report results over multiple random seeds and assess thinking quality with independent evaluation metrics?
3 comments

We sincerely thank you for your careful review and valuable comments. Below, we provide point-by-point responses to each comment.

W1 and Q1: Regarding RLVR-to-GQA transfer

R: We agree that the original results provide only indirect evidence regarding transfer. We therefore evaluated the Qwen3-1.7B model before and after MATH-GRPO training (Table 2, Setting C) on ExpertQA, pairing its post-training thinking traces with the base answering model (Tpost+ApreT_{post}+A_{pre}).

ConfigurationRewardWin Rate (vs. Base)
Qwen3-1.7B0.1842-
Tpost+ApreT_{post} + A_{pre}0.183745.54%
Tpre+ApostT_{pre} + A_{post}0.184451.59%
Post-trained0.184049.17%

The Tpost+ApreT_{post}+A_{pre} configuration does not outperform the base model (45.54% win rate), nor does the full post-trained model (49.17%). Thus, thinking learned through MATH RLVR does not transfer into improved GQA performance. We have added these results to the revised appendix.

W2 and Q2: Regarding the Rationale for Phase I

R: We thank the reviewer for highlighting this distinction. Because thinking and answering share parameters, masking answer tokens removes their direct policy-gradient contribution but does not freeze the answering policy. We have therefore replaced the inaccurate terms “fixed,” “stationary,” and “solely” with the more precise statement that Phase I focuses direct optimization on thinking tokens.

Although answer tokens are excluded from the loss, thinking-token gradients still update the shared parameters, indirectly changing the answer distribution. This explains the +0.0055+0.0055 gain for Tpre+ApostT_{pre}+A_{post} in Table 5. More importantly, Tpost+ApreT_{post}+A_{pre} improves by +0.0046+0.0046 (69.11% win rate) with the unchanged base answerer, compared with only +0.0007+0.0007 (52.87%) under direct RL in Table 1. Thus, Phase I nevertheless improves the standalone utility of thinking traces.

Q3: Regarding Ablations with Thinking-Only Training and a Truly Frozen Answering Policy

R: Phase I already restricts direct optimization to thinking tokens. However, because thinking and answering share parameters, any update to the thinking policy may also change the answer distribution. Implementing a truly frozen answering policy would require a separate frozen answerer or explicitly disentangled parameters, which would change the architecture and training pipeline and make a matched comparison difficult. As a controlled alternative, Table 5 fixes the answerer at evaluation, showing that Phase-I thinking traces improve reward by +0.0046+0.0046 with a 69.11% win rate when paired with the unchanged base answerer.

Q4: Regarding random seeds and independent evaluation metrics for thinking

R: Repeating large-scale RL post-training with multiple training seeds incurs substantial computational cost. We instead evaluated the main checkpoints from Table 3 with three inference seeds (mean ±\pm standard deviation):

Config.Post-trained RewardPost-trained Win RateTpost+ApreT_{post} + A_{pre} RewardTpost+ApreT_{post} + A_{pre} Win Rate
GRPO0.2173 ±\pm 0.0008—0.1847 ±\pm 0.0005—
GRPO-MA0.2135 ±\pm 0.000432.80% ±\pm 1.19%0.1848 ±\pm 0.000848.30% ±\pm 4.37%
+START0.2219 ±\pm 0.001371.02% ±\pm 8.50%0.1868 ±\pm 0.000662.10% ±\pm 4.33%

Rewards remain stable, while win rates show larger variation; nevertheless, the qualitative ranking is preserved across inference seeds.

Regarding independent thinking metrics, directly assessing open-domain thinking is currently infeasible because there is no established intrinsic metric. This is precisely why we introduce Cross-Generation: it evaluates the functional contribution of a thinking trace by pairing it with the same answering model, rather than relying on subjective direct scoring.

Reviewer_qJeROpenReview ↗

Response to Authors

Thank you for the detailed response and additional experiments. However, several key concerns remain unresolved. First, the RLVR-to-GQA transfer experiment is limited to a single setting, which is insufficient to support the broad conclusion. Second, the proposed mechanism still lacks a controlled ablation with a truly frozen answering policy. Third, inference-seed evaluations cannot replace multiple training seeds, and independent evidence of improved thinking quality remains missing. Therefore, I maintain my original rating.

We thank the reviewer for the continued discussion and for these constructive comments.

On the RLVR-to-GQA Transfer Experiment

R: We would like to clarify the role of this experiment and the scope of our claim. Our conclusion is that "RL training on GQA does not directly improve thinking ability", and it does not rest on the transfer experiment alone: Table 1 reports six GQA settings (three model scales, two algorithms, three datasets) in which Tpost+ApreT_{post}+A_{pre} gains are negligible. The MATH-RLVR experiment addresses a narrower question — whether thinking learned from verifiable rewards transfers into GQA — and its negative answer supports why GQA-specific RL is necessary. We agree that this experiment covers one model/task pair, and we state this scope explicitly in the appendix; it is supporting evidence, not the sole basis for the conclusion.

On the Frozen Answering Policy

R: We would like to clarify that such an ablation is not well-defined under a shared-parameter architecture: because thinking and answering are produced by the same parameters, any update from thinking tokens necessarily alters the answer function. We therefore instantiate this control at evaluation time. In Tpost+ApreT_{post}+A_{pre} (Table 5), the answerer is fixed to the base model and the thinking trace is the only varying factor, which directly isolates the claim: Phase I does improve thinking quality.

On Training Seeds and Independent Evidence of Thinking Quality

Seeds. We would like to clarify that training-seed replication is not standard in this literature (e.g., GRPO [1] and DAPO [2] both only report single training runs), and is hardly feasible considering the rebuttal period. We instead used three inference seeds; the resulting variation (≤8.5 points) is well below START's margins over the strongest baseline (13.8 and 38.2 points), and the ranking is preserved.

Thinking quality. While no dedicated metric exists, Cross-Generation offers a controlled functional measure: with the answerer fixed, Tpost+ApreT_{post}+A_{pre} isolates the trace's contribution. START improves this measure from 54.14% to 68.15% win rate (Table 3), with the same ordering under the independent Llama3-70B judge (59.23% vs. 49.68%)(additional experiment suggested by Reviewer LcQd). As the same measure also revealed thinking stagnation in Section 3, this gain directly demonstrates an improvement in thinking quality.

Table 3, Llama3-70B judge (win rate vs. post-trained GRPO):

Config.Post-trainedTpost+ApreT_{post}+A_{pre}
GRPO——
GRPO-MA45.22%49.68%
+START52.23%59.23%

Table 4, Llama3-70B judge (START vs. the respective vanilla post-trained baseline):

SettingSTART Win Rate
ExpertQA / Qwen3-1.7B / DAPO56.41%
UltraFeedback / Qwen3-1.7B / GRPO53.75%
AlpacaEval / Qwen3-1.7B / GRPO52.05%
ExpertQA / Hunyuan-1.8B / GRPO56.05%
ExpertQA / Qwen3-4B / GRPO54.14%

References

[1] Shao, Z., Wang, P., Zhu, Q., Xu, R., Song, J., Bi, X., et al. DeepSeekMath: Pushing the Limits of Mathematical Reasoning in Open Language Models. arXiv preprint arXiv:2402.03300, 2024.

[2] Yu, Q., Zhang, Z., Zhu, R., Yuan, Y., Zuo, X., Yue, Y., et al. DAPO: An Open-Source LLM Reinforcement Learning System at Scale. Advances in Neural Information Processing Systems 38 (NeurIPS), 2025.

Reviewer_LcQdOpenReview ↗
Rating
3
Confidence
4
Informativeness
2
Presentation
2
Soundness
3
Read review
Paper summary

The paper asks whether the thinking ability elicited by RLVR transfers to general QA (GQA). The authors propose a Cross-Generation evaluation that pairs the thinking trace of one model with the answering stage of another. Using it, they argue that (i) thinking matters much less for GQA than for MATH, and (ii) RL directly on GQA mostly improves the answer while the thinking barely changes ("thinking stagnation"). To address this, they propose START. In the first stage, gradients on answer tokens are masked so that only thinking tokens are updated; the second stage is standard joint RL. Experiments on ExpertQA, UltraFeedback and AlpacaEval with Qwen3/Hunyuan models and GRPO/DAPO show consistent gains over the vanilla baselines.

Critical strengths
  1. The question is relevant and under-explored. It is often assumed that reasoning gains from RLVR carry over to open-ended tasks, and this paper actually tries to measure it.

  2. START is interesting and very easy to adopt: a token-level loss mask that plugs into existing GRPO/DAPO pipelines at no extra cost.

Critical weaknesses

Critical Weaknesses:

  1. The judge behind most win rates is not specified. Apart from the AlpacaEval LC numbers in Section 2.1 (Llama3-70B judge), the paper does not say who decides the win rates in Tables 1–6 and 10. Several entries are exactly 100% on a test set of roughly 157 prompts. That is hard to get from an LLM judge, but easy if the training reward model (ArmoRM) is also the judge. If so, the gains of START could partly reflect reward over-optimization rather than better outputs. The independent judge from Section 2.1 is already set up, so it seems natural to use it for the START results too.

  2. The title claim is not directly tested. The only RLVR runs in the paper (Table 2 Setting C, Table 11) are trained and evaluated on MATH. Section 2.1 compares off-the-shelf Qwen3 models of different sizes, so the varying factor is model scale, not RLVR. The experiment that would support the title is missing: plug thinking traces from a MATH-RLVR model into GQA and compare them with pre-RLVR traces.

  3. Related work. Answer-span gradient masking in GRPO, motivated by a very similar shortcut argument, appears in the recent concurrent work OM-GRPO ("Don't Peek at the Answer", arXiv 2608.03119) [1]. VeriFree (ICLR 2026) [2] also optimizes only the reasoning, against a truly fixed reference answer. A short discussion would help clarify what is specific to START, e.g., the GQA diagnosis and the two-stage schedule.

References

[1] Yongshi Ye, Liang Zhang, Yidong Chen, Xiaodong Shi, and Biao Fu. Don't Peek at the Answer: Outcome-Masked Group Relative Policy Optimization for Label-Free RLVR. arXiv:2608.03119, 2026.

[2] Xiangxin Zhou, Zichen Liu, et al. Reinforcing General Reasoning without Verifiers. In ICLR, 2026. arXiv:2505.21493.

Questions for authors
  1. Evaluation judge. Who determines the win rates in Tables 1–6 and 10: ArmoRM scores, or an LLM judge? Could you report the main START vs. GRPO comparison (Table 3 and Table 4) using the AlpacaEval LC setup with the Llama3-70B judge from Section 2.1?

  2. Testing the title claim. Could you take the MATH-RLVR model from Table 2 Setting C, pair its thinking traces with the base answerer on ExpertQA or AlpacaEval, and compare against the base thinking traces? This would directly show whether RLVR-trained thinking transfers to GQA.

3 comments

We sincerely thank you for your careful review and valuable comments. Below, we provide point-by-point responses to each comment.

W1 and Q1: Regarding the Judge Used for Most Win Rates

R: Thank you for identifying this ambiguity. For the GQA experiments, the win rates in Tables 1-6 were computed from pairwise ArmoRM scores; Table 10 instead used Skywork-Reward-V2-Qwen3-8B. We have clarified the evaluators in the revised text.

We agree that evaluation with the training reward model cannot by itself exclude reward over-optimization. These results serve primarily as a controlled Cross-Generation diagnostic of whether reward gains arise from thinking or answering. We therefore re-evaluated Tables 3 and 4 using the independent Llama3-70B judge from Section 2.1. For Table 3, the win rates against post-trained GRPO are:

Config.Post-trainedTpost+ApreT_{post} + A_{pre}
GRPO--
GRPO-MA45.22%49.68%
+START52.23%59.23%

For Table 4, START's win rates against the respective vanilla post-trained baselines are:

SettingSTART Win Rate
ExpertQA / Qwen3-1.7B / DAPO56.41%
UltraFeedback / Qwen3-1.7B / GRPO53.75%
AlpacaEval / Qwen3-1.7B / GRPO52.05%
ExpertQA / Hunyuan-1.8B / GRPO56.05%
ExpertQA / Qwen3-4B / GRPO54.14%

Although the independent-judge margins are more moderate, START remains above 50% in all five settings and reaches 59.23% for Tpost+ApreT_{post}+A_{pre} in Table 3. Thus, the gains are not limited to the training reward model. We have added these results to the revised appendix.

W2 and Q2: Regarding the Title Claim "RLVR TRAINING OF LLMS ..."

R: To directly test RLVR-to-GQA transfer, we evaluated the Qwen3-1.7B model post-trained on MATH with GRPO (Table 2, Setting C) on ExpertQA. We paired its post-training thinking traces with the base answering model (Tpost+ApreT_{post}+A_{pre}), as suggested by the reviewer.

ConfigurationRewardWin Rate (vs. Base)
Qwen3-1.7B0.1842-
Tpost+ApreT_{post} + A_{pre}0.183745.54%
Tpre+ApostT_{pre} + A_{post}0.184451.59%
Post-trained0.184049.17%

The Tpost+ApreT_{post}+A_{pre} configuration does not outperform the base model (45.54% win rate), nor does the full post-trained model (49.17%). This provides direct evidence that thinking learned through MATH RLVR does not transfer into improved GQA performance. We have added these results to the revised appendix.

W3: Regarding Related Work

R: Thank you for highlighting these related works. They study settings distinct from ours: OM-GRPO addresses mode collapse in majority-voting-based label-free RLVR, while VeriFree assumes a fixed reference answer and directly optimizes its tokens through a reward-weighted supervised term. In contrast, START targets open-ended GQA with no fixed reference answer.

OM-GRPO nevertheless shares the principle of removing direct answer-token gradients. START further differs by diagnosing thinking stagnation through Cross-Generation and adopting a two-stage schedule that first directs optimization toward thinking tokens and then jointly optimizes thinking and answering. We have clarified these connections and distinctions in the revised Related Work.

Thank you for your response. I will maintain my original score.

Thank you for your feedback. We greatly appreciate your careful evaluation and constructive suggestions. If you have any further questions, please feel free to contact us!

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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