acceptodds
Under review as a conference paper at ICLR 2027

Prefix-Balanced Decoding: Optimal Occupancy under Causal Coupling

Abstract

Correlated autoregressive samples can improve coverage without changing each completed sample’s marginal. That guarantee need not survive inspection of the partial batch: other lanes may reveal shared randomness and distort a selected lane’s next-token law. We study couplings that preserve every named lane’s conditional given the full public history. Prefix-balanced decoding (PBD) meets this contract by refreshing a systematic categorical coupling within exact-prefix groups. We prove that one target-free process minimizes every individual prefix count in convex order, over all history-adapted admissible couplings. More strongly, local floor/ceiling counts characterize all such universal optimizers; minimizing one positive weighted sum of prefix-count variances is sufficient to identify this entire class. A Bellman gap identity, a conditional restart theorem, and two ordering results explain the mechanism: more balancing improves occupancy on a fixed tree, whereas exposing a finer factorization can worsen the causal optimum. On finite intent decoders induced by three real language models, PBD improves pass@8 by 1.116 percentage points, recovers 99.5% of the endpoint-aligned opportunity, and retains 98.7% of the gain with four balanced levels. Under a shared adaptive budget, full PBD also improves target-free pass by 1.09 percentage points. These results connect an exact characterization of sampling dependence to effective shallow coordination under an inspection-stable contract.

Primary area:
learning theory
Keywords:
prefix-balanced decoding, correlated sampling, causal coupling, convex order, occupancy optimization, autoregressive decoding, diverse decoding, language models

Reviews

Among:
Shape:
1234this paper, Bottom 49%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.25 over 4 reviews, above 49% of the others.
Reviewer_sNWXOpenReview ↗
Rating
1(−1)
Confidence
3
Informativeness
3
Presentation
2
Soundness
2
Read review
Paper summary

The paper proposes prefix-balanced decoding, which coordinates samples within identical-prefix groups while preserving each sample’s next-token distribution conditional on the full observed batch history. It characterizes optimal prefix occupancy under this constraint and reports consistent but modest gains on finite intent decoders derived from three language models.

Critical strengths
  1. The distinction between endpoint marginal validity and validity conditional on the observed batch is clearly formulated. Theorems 1–2 provide a useful characterization of all universal prefix-occupancy optimizers, going beyond the classical one-step balancing construction.

  2. The finite-decoder experiments isolate the effect of sampling dependence by using identical model posteriors and exact static occupancy calculations. The paired uncertainty analysis and explicit discussion of the method’s limitations make the reported results reasonably convincing within this setting.

Critical weaknesses
  1. The practical importance of the stronger conditional-validity requirement remains unclear. The endpoint lattice’s post-inspection TV discrepancy (0.00236) and target-calibration gap (0.00143) are both below the prespecified 0.01 materiality threshold, and the experiments do not show that these discrepancies cause a consequential downstream error (section 5.1, table 16).

  2. The optimality guarantees concern individual prefixes and separable occupancy objectives; they do not cover arbitrary semantic sets of correct answers, and the restart theorem only establishes optimal continuation after a single selection at a common state. The canonical-label experiments closely match these assumptions, leaving the significance of the results for broader adaptive generation insufficiently established (proposition 2, theorem 5).

  3. The roughly one-percentage-point gains are reported without measuring the cost of prefix grouping and synchronized decoding. Since the evaluation uses precomputed finite-label posteriors, it remains unclear whether these gains translate into a useful improvement at a fixed runtime budget.

The characterization is useful, but I am not convinced that its significance within the stated setting, together with the current empirical evidence, is sufficient for acceptance. I recommend weak rejection because the need for the stronger contract and its practical value remain insufficiently demonstrated, rather than because of an identified error in the main proofs.

Questions for authors
  1. Can the authors show whether the measured conditional distortions change a downstream selection or budget-allocation decision? Given that the reported discrepancies are below the materiality threshold, a concrete decision-level effect would strengthen the motivation for the stricter contract.

  2. Could the authors examine a small extension of the finite-decoder experiment in which several output strings count as successful, rather than a single canonical label? In light of Proposition 2, this would help determine whether the observed benefits survive a modest relaxation of the evaluation assumptions.

  3. Could Full PBD, PBD4, IID, and the endpoint-lattice references be compared on the same 1,368-row integration subset, with paired utility differences? As appendix D.4 acknowledges, the reported primary PBD and lattice averages use different query populations and therefore do not establish a direct comparison.

  4. What runtime overhead do prefix grouping and synchronization introduce relative to iid decoding? A comparison of IID, PBD4, and Full PBD under a matched time budget would help establish whether shallow coordination offers a useful practical tradeoff.

If the authors can satisfactorily address the above questions and clarify the practical cost-benefit tradeoff of the proposed method, I would be open to raising my rating.

6 comments
AuthorsOpenReview ↗

Weakness 1 and Question 1, decision consequences

Thank you for recognizing that Theorems 1–2 go beyond classical one-step balancing and that the controlled paired evaluation is informative. We answer Questions 1–4 in your order, naming the overlapping weaknesses explicitly. This comment addresses Q1; the next covers Q2 and the remainder of Weakness 2; the final comment covers Q3 and Q4.

Weakness 1 and Question 1: Do the measured conditional distortions change a decision?

Thank you for asking us to connect conditional fidelity to an actual decision. We have added a controlled equal-budget example in which the conditional interface changes the appropriate selection and its success probability. For the unchanged consumer, success increases from 1/4 under endpoint coupling to 1/3 under PBD.

Let P(A0,A1,B0,B1)=(1/4,1/2,1/16,3/16), with success {A0,B0}. Two lanes reveal their first tokens, and one is retained for its last token. The base selector prefers A, with success probability 1/3, to B, with probability 1/4. Every policy spends three transitions.

The endpoint lattice S and (S+1/2) mod 1, with S uniform, has the same observed-history probabilities as PBD: AA, AB, and BA occur with probabilities 1/2, 1/4, and 1/4. In mixed endpoint histories, the A lane's actual success probability is zero. The unchanged selector consequently achieves 1/4, whereas PBD preserves the retained A lane's conditional success probability of 1/3. A selector that explicitly recalibrates instead chooses B on mixed histories and achieves 3/8. The example therefore shows both the consequence of reusing the unchanged conditionals and the valid endpoint-aware alternative.

We distinguish this controlled mechanism from its prevalence in the measured population. The short-label mean TV is 0.00236, and the oracle-selected calibration gap is 0.00143; those measurements do not themselves isolate a consequential real-query decision change. The prespecified 0.01 criterion applies to mean TV, not to a separately specified calibration-gap criterion.

Section 2 (p. 3) now states the consumer, and Appendix F.1, Table 19 (p. 27), provides the calculation. Section 5.1 (p. 8) and Appendix D.4 (pp. 24–25) separate fidelity measurements from decision regret. Our Q3 reply adds the complementary real-query utility comparison under a common controller, without attributing its difference to distortion alone. Together, these additions make the motivation concrete while keeping the decision mechanism and empirical comparison distinct.

AuthorsOpenReview ↗

Weakness 2 and Question 2, multiple correct strings

Weakness 2 and Question 2: Do the benefits survive several successful strings?

Thank you for proposing this specific extension. Yes, full PBD improves the mean in all six tested model–dataset settings. We newly score the canonical phrase and two natural paraphrases per intent, including EOS, and evaluate success on their union. The study uses the same 7,610 distinct inputs across three fixed checkpoints: 3,080 BANKING77 and 4,530 primary CLINC queries per model, giving 22,830 model–query evaluations.

ModelBANKING77 gainCLINC gain
Phi-3.5-mini+1.18 pp+1.47 pp
Qwen2.5-3B+1.09 pp+1.11 pp
Qwen2.5-7B+0.84 pp+0.65 pp

The equal-cell full-PBD minus IID gain is 1.06 percentage points, paired 95% interval [1.00, 1.11], and multiplicity-adjusted 98.33% interval [0.99, 1.13]. Absolute semantic hit is 69.67%/70.72%/70.73% for IID/PBD4/full PBD. Token-order and class-contiguous endpoint references attain 70.740%/70.742%, under their distinct contracts. PBD4 retains 99.3% of the full gain.

All methods use identical query identities and newly scored posteriors. The PBD calculation integrates joint sibling allocations for the correct-string union rather than adding singleton hit probabilities. Query resampling is stratified within intents and shared across models and methods, so repeated model evaluations do not become independent inputs.

The catalog was fixed before scoring. Canonical strings retain 99.4% of normalized mass, and the same-prompt canonical-only control gives a 1.06-point gain. The result therefore supports the modest relaxation you requested: the aggregate benefit survives several naturally scored successful strings, while Proposition 2's boundary for arbitrary semantic unions remains unchanged. Section 5.2 (p. 9) and Appendix F.2, Tables 20–21 (p. 28), report the complete comparison and control.

Weakness 2, continued: Does the restart theorem cover broader adaptive generation?

We appreciate this distinction. A related reviewer request motivated a repeated reward-guided pruning study, which also addresses this part of your concern. We evaluated 94,968 requests on GSM8K using a frozen, gold-free Qwen2.5-Math-PRM-7B controller, retaining four unfinished lanes at depth 64 and two at depth 192. Controller cost is included, and unpruned controls retain the verifier.

The primary timed full-PBD minus IID effect is −0.44 points, adjusted interval [−1.52, 0.66], so the study does not establish a utility ordering in this setting. Section 5.4 (p. 10) and Appendix F.4 (p. 30) report all fixed schedules and the matched-block configuration mixture. This supplies the broader controller evaluation rather than assuming its performance follows from Theorem 5, whose guarantee remains completion from the same once-selected state without further pruning.

AuthorsOpenReview ↗

Question 3 and Weakness 3 / Question 4, matched comparisons

Question 3: Can all five methods be compared on the identical 1,368-row subset?

Thank you for identifying the population mismatch. We now compare all five methods on exactly the same 1,368 model–query rows, representing 456 distinct queries from the canonical-label experiment. The settings are T=1, initial K=8, observation depth two, retained budget four, and the same target-free controller.

MethodTarget-free pass (%)
IID67.837
PBD468.879
Full PBD68.880
Token-order endpoint lattice68.776
Label-order endpoint lattice68.758

Full PBD exceeds the token-order lattice by 0.104 percentage points [0.009, 0.202] and the label-order lattice by 0.122 points [0.020, 0.225]. These post-hoc descriptive 95% intervals resample queries within intents, preserve pairing across models and methods, and condition on the stored boundary estimates.

Section 5.1 (p. 9) displays the common-population means; Appendix F.5, Tables 26–27 (p. 31), gives all paired utility differences. This resolves the denominator concern and provides the requested direct comparison. Its scope is a common-controller, common-budget comparison, rather than an equal-time result or causal attribution to distortion.

Weakness 3 and Question 4: What is the coordination cost at a matched time budget?

Thank you for asking for an actual runtime comparison rather than an operation count. We evaluated all 1,319 GSM8K test questions, four randomizations, Qwen2.5-7B-Instruct, K=8, and a 1,024-token cap. The 31,656 requests include fixed-K and genuine deadline-limited trials.

MethodFixed-K median latencySuccess by the 9.31 s deadline
IID6.39 s96.38%
PBD46.40 s96.38%
Full PBD6.74 s96.10%

PBD4's median is approximately 0.2% above IID, calculated before rounding, and both have the same observed deadline-success estimate. Their paired difference is 0.00 points, adjusted 98.33% interval [−0.53, 0.55]. The full-PBD timed difference is −0.28 points, nominal 95% interval [−0.70, 0.13]. These quantify the tradeoff directly; observed closeness does not establish superiority or formal equivalence.

The deadline was fixed from training-only timing. Methods share model/cache paths and instrumentation in matched execution blocks. An output must finish or reach the cap, satisfy the frozen final-line parser, and be available before the deadline. Randomizations are averaged within question before paired question-cluster resampling. The measurements cover complete-request cost, not isolated grouping or synchronization components.

Section 5.3 (pp. 9–10) and Appendix F.3, Tables 22–23 (p. 29), report these results. Combined with PBD4's 99.3% gain retention in the separate multi-phrase workload, they make the shallow-coordination case concrete. We respectfully ask you to reconsider your assessment in light of the positive semantic extension, corrected paired comparison, explicit decision example, and measured cost–benefit profile.

Thank you for your time and effort.

Reviewer_qZEuOpenReview ↗
Rating
3(+1)
Confidence
2
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper studies sampling approaches that can improve coverage that preserve every named lane’s conditional given the full public history, this is more strict constraints compared to previous correlated autoregressive samples which maintains each completed sample’s marginal. This paper proposes Prefix-balanced decoding (PBD) that meets the required constraints and proves that one target-free process minimizes every individual prefix count in convex order, over all history-adapted admissible couplings. Experiments show that PBD improves pass@8 by 1.116 percentage points and retains 98.7% of the gain with four balanced levels.

Critical strengths

The theoretical part is interesting and new. In section 2, this paper clearly introduces the constraints, Public-history causal validity, then the goal, minimizing every individual prefix count in convex order, and the proposed algorithm, Prefix-balanced decoding. In section 3, it demonstrates the optimum of PBD, local balance remains globally optimal.

The proposed PBD is simple but effective.

Critical weaknesses
  1. I think the main weakness of this paper is the necessity of the motivation is not significant. Improving coverage without changing each completed sample’s marginal is enough for most scenarios, why it is necessary to preserve every named lane’s conditional given the full public history?

  2. The experiments are limited and the results are moderate. For instance, the proposed PBD algorithm doesn't achieves better pass@8 compared to previous correlated autoregressive sampling methods.

Questions for authors

Could the authors provide scenarios requiring post-inspection conditional fidelity?

4 comments
AuthorsOpenReview ↗

Weakness 1 and Question 1, why the contract matters

Thank you for recognizing the theoretical result as interesting and new, and the method as simple and effective. We address your first weakness together with your question about a scenario requiring post-inspection fidelity, then turn to the experimental comparison.

Weakness 1 and Question 1: Why preserve conditionals after inspecting the whole batch?

We appreciate the request for a concrete consumer. The contract supports a controller that inspects partial generations, then uses the decoder's original prefix probabilities to decide which continuations receive the remaining budget. Endpoint validity alone does not keep this unchanged probability interface correct after other lanes have been observed. We agree that consumers using only completed samples may need only the weaker endpoint guarantee.

Let P(A0,A1,B0,B1)=(1/4,1/2,1/16,3/16), with success event {A0,B0}. Observe two first tokens and retain one lane for its final token. Since the base success probabilities are 1/3 from A and 1/4 from B, the unchanged consumer chooses A whenever available. Each policy uses exactly three transitions.

For the endpoint lattice S and (S+1/2) mod 1, with S uniform, histories AA, AB, and BA occur with probabilities 1/2, 1/4, and 1/4, exactly as under PBD. On mixed endpoint histories, the A lane's actual success probability is zero despite its base value 1/3. The unchanged consumer therefore succeeds with probability 1/4 under endpoint coupling versus 1/3 under PBD. Both the observation law and transition budget are controlled.

An endpoint-aware consumer can explicitly recalibrate, choose B on mixed histories, and achieve 3/8. This is a valid alternative under a different conditional interface. PBD gives the exact individual-prefix occupancy optimum while preserving the reusable original interface; it does not require a downstream consumer to reconstruct the coupled posterior.

What the revision clarifies. Section 2 (pp. 2–3) defines the available information and now places this example immediately before the construction and optimum. Appendix F.1, Table 19 (p. 27), gives all three outcomes. This makes the motivation explicit: the stronger requirement is useful when the original conditional interface is part of the consumer's requirements. The paper then solves that constrained problem exactly and characterizes every universal optimizer, rather than merely proposing one method that satisfies it.

AuthorsOpenReview ↗

Weakness 2, experimental scope and endpoint comparisons

Weakness 2: Limited experiments, moderate gains, and comparison with endpoint sampling.

Thank you for asking how the empirical evidence supports the value of the stronger contract. The revision now supplies three complementary comparisons.

Multiple correct strings. A related request from another reviewer motivated the multi-phrase experiment, which also addresses your concern about empirical scope. Full PBD achieves 70.73% semantic hit versus IID's 69.67%, a gain of 1.06 points, with adjusted 98.33% interval [0.99, 1.13] and positive means in all six settings. It is only 0.012 points below the class-contiguous endpoint reference's 70.742%.

That reference changes the public factorization and operates under a weaker contract. Its slightly higher static coverage is therefore compatible with PBD's constrained prefix optimum: the comparison measures the coverage price of retaining the original conditional interface. This semantic result is empirical, not a semantic-union theorem; canonical phrases retain 99.4% of normalized mass.

A direct adaptive comparison. Another reviewer asked that all methods use identical inputs. This is also relevant to your endpoint-baseline concern. On the same 1,368 model–query rows, full PBD exceeds the token-order endpoint lattice by 0.104 points [0.009, 0.202] in target-free success. The comparison uses a common controller and retained budget, with post-hoc nominal 95% paired intervals conditional on boundary estimates. It establishes a direct utility comparison in this setting, not a causal isolation of fidelity or a reproduction of complete prior online systems.

Online generation and shallow coordination. We also evaluated full-vocabulary GSM8K generation on all 1,319 test questions with four randomizations. PBD4's fixed-K median is 6.40 s versus IID's 6.39 s, approximately 0.2% higher before rounding. Both achieve 96.38% success by the fixed 9.31 s deadline; the paired difference is 0.00 points, adjusted interval [−0.53, 0.55]. A usable answer must satisfy the frozen final-line parser and finish or reach the cap before the deadline. These online measurements complement PBD4's 99.3% retention of the multi-phrase gain in the separate finite-inventory study.

Where the changes appear. Section 5.2 and Appendix F.2 (pp. 9 and 28) give the semantic comparison; Section 5.1 and Appendix F.5 (pp. 6–9 and 31) give the matched adaptive comparison; Section 5.3 and Appendix F.3 (pp. 9–10 and 29) report online cost and success.

Together with the concrete consumer in our first reply, these additions establish a clearer reason for the constraint and quantify its empirical tradeoff. We respectfully invite you to reconsider the significance of the exact characterization on this strengthened evidence.

Thanks again for your time and effort.

Thank you for the detailed response. The motivating example and additional experiments partially address my concerns, it better establish the usefulness of PBD in settings that require post-inspection conditional fidelity. However, the evidence for broader practical significance remains limited. I therefore continue to view the paper’s primary contribution as its theoretical characterization. In recognition of the clarified motivation and strengthened empirical evidence, I will raise my score to 3.

Thank you for taking another look at our paper and for raising your recommendation to Weak Accept. We appreciate the time you spent examining the motivating example and the additional results, and we are glad they helped clarify when the conditional guarantee is useful.

Your question about the intended consumer helped us make the motivation more concrete. The central contribution is the exact characterization of optimal individual-prefix occupancy while preserving each lane's original next-token conditionals after the partial batch is inspected. The finite-decoder results provide supporting evidence in the tested settings. We appreciate your recognition of this theoretical contribution and your emphasis on keeping the practical claims tied to the evidence.

Thank you again for the constructive discussion and for reconsidering your assessment. Your feedback helped us explain more clearly how the conditional requirement, the intended use case, and the empirical results fit together.

Reviewer_Z1RuOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper proposes Prefix-Balanced Decoding (PBD), a sampling strategy designed to improve diversity across multiple autoregressive generations while preserving each sample's conditional next-token distribution, even when other generated prefixes are observed. The method groups samples sharing the same prefix and uses systematic categorical sampling to balance their allocation across possible next tokens.

Critical strengths
  1. Strong theoretical contributions: The paper provides rigorous mathematical guarantees for prefix occupancy optimization, including a characterization of all universally optimal sampling strategies. The analysis establishes a meaningful connection between local balancing decisions and globally optimal prefix-count distributions.

  2. Preservation of conditional sampling distributions: Unlike diversity-promoting decoding methods that alter the underlying sampling distribution, PBD maintains each named sample's conditional next-token distribution after the complete public history is observed. This is an interesting property for applications involving adaptive sampling and selective continuation.

  3. Computationally attractive shallow balancing: The observation that balancing only the first four decoding levels retains 98.7% of the improvement is promising. This suggests that much of the benefit can be achieved without coordinating the entire generation process.

  4. Consistent experimental improvements: The method improves pass@8 across all six model–dataset combinations and multiple temperature and batch-size settings. The authors also evaluate additional diversity metrics, including distinct outputs, entropy, and collisions, which generally support the theoretical predictions.

  5. Analysis of adaptive sampling: The paper considers scenarios where a controller observes partial generations and selectively continues a subset of samples. This extends the contribution beyond conventional parallel sampling and provides additional motivation for maintaining conditional distribution correctness.

Critical weaknesses
  1. Limited evaluation on real-world generation tasks: The experiments are restricted to intent classification datasets, where the output space consists of a finite inventory of labels. This is considerably simpler than open-ended language generation, where the vocabulary is large and trajectories can be arbitrarily long. Experiments on mathematical reasoning, code generation, or other open-ended generation tasks would substantially strengthen the paper's practical relevance.

  2. Relatively small practical improvements: Although statistically consistent, the average pass@8 improvement of 1.116 percentage points is modest. Furthermore, the reported 99.5% recovery of the endpoint-aligned opportunity measures improvement relative to a limited achievable gain rather than overall task performance. The practical significance of these improvements needs stronger justification.

  3. Unclear scalability and inference overhead: PBD requires grouping samples by exact prefixes, synchronizing decoding steps, and coordinating token sampling. The experiments use finite label inventories for which complete sequence probabilities can be computed in advance. It remains unclear how efficiently the method can operate with standard autoregressive decoding over large vocabularies. Runtime, memory, and throughput comparisons against independent sampling would be valuable.

  4. Limited comparison with existing correlated sampling methods: The paper discusses Arithmetic Sampling and quasi-random sampling approaches but does not provide comprehensive experimental comparisons with their existing implementations on realistic generation tasks. The endpoint-aligned baseline is useful theoretically, but stronger empirical comparisons would help establish PBD's practical advantages. Moreover, the measured conditional-distribution violations of the endpoint baseline are relatively small, raising questions about the practical importance of enforcing exact conditional validity.

  5. The theoretical guarantees do not necessarily translate to semantic diversity: The optimality results apply to individual prefix counts and separable occupancy objectives, rather than arbitrary semantic diversity or downstream utility functions. The authors themselves provide examples where universally optimal prefix-count samplers can perform worse than independent sampling on semantic-set coverage. Consequently, improved prefix diversity does not necessarily guarantee more useful or semantically diverse generations.

  6. Restricted adaptive evaluation: The adaptive experiments consider a specific setting where eight samples are generated, four are retained after two decoding steps, and the retained samples are completed without further pruning. Real-world adaptive search algorithms may involve repeated pruning, dynamic budget allocation, and reward-guided selection. Evaluating PBD in such settings would better establish its usefulness for practical inference-time search.

Questions for authors

Answer the weakness for the questions above.

4 comments
AuthorsOpenReview ↗

Weaknesses 1–3, generation, effect size, and cost

Thank you for recognizing the optimizer characterization, conditional preservation, consistent finite-decoder gains, and promise of shallow coordination. The added studies directly examine that promise. We follow your six concerns in order, with Weaknesses 1–3 here and Weaknesses 4–6 in the companion comment.

Weakness 1: Evaluation beyond finite intent inventories.

We agree that ordinary generation is needed to assess relevance beyond precomputed labels. We therefore evaluated full-vocabulary GSM8K generation with Qwen2.5-7B-Instruct on all 1,319 test questions, using four randomizations, K=8, and a 1,024-token cap. The 31,656-request study covers fixed-K and actual deadline-limited trials. Under the training-calibrated 9.31 s deadline, IID and PBD4 both achieve 96.38% usable-answer success; full PBD achieves 96.10%. The primary PBD4 minus IID difference is 0.00 points, adjusted 98.33% interval [−0.53, 0.55].

This adds a complete open-output reasoning workload and measures the practical comparison directly. Success requires a completed or capped answer satisfying the frozen final-line numeric parser and, in timed trials, availability before the deadline. Section 5.3 (pp. 9–10) and Appendix F.3 (p. 29) state this endpoint and uncertainty. The completed scope is one online model and reasoning benchmark; code generation is not included.

Weakness 2: Absolute effect size and the interpretation of opportunity recovery.

Thank you for distinguishing task accuracy from recovery of available headroom. We report both. The canonical-label gain is 1.116 percentage points, against approximately 1.121 points of endpoint headroom. Thus 99.5% recovery quantifies how little available coverage is sacrificed for the stronger conditional interface, not a percentage increase in overall accuracy.

The new multi-phrase study extends this evidence: all six setting means improve, by 0.65 to 1.47 points. The equal-cell gain is 1.06 points, adjusted interval [0.99, 1.13]; PBD4 gives 1.05 points, retaining 99.3% of the full gain. Table 1 (p. 6) and Appendix F.2 (p. 28) report the absolute comparisons. The original 0.986-point four-Qwen estimate narrowly missed its prespecified 1-point criterion; Appendix B.2 (p. 19) preserves that separate decision.

Weakness 3: Scalability, grouping cost, memory, and throughput.

We appreciate the request for systems measurements. The online implementation uses next-token probabilities at occupied prefixes, without enumerating complete sequences. Fixed-K median latencies are 6.39/6.40/6.74 s for IID/PBD4/full PBD; corresponding p95 values are 10.86/10.75/11.58 s. PBD4's median is approximately 0.2% higher than IID, calculated before rounding.

Methods share execution, precision, cache management, compaction, and instrumentation within matched blocks. These results directly answer complete-request latency and deadline utility; grouping-only cost, peak-memory scaling, and production throughput are separate quantities not established by this comparison. Appendix F.3, Tables 22–23 (p. 29), and Supplement S.1 explain the measurement design. The practical finding is that the shallow variant operates at nearly IID median latency, complementing its retention of nearly all measured multi-phrase benefit in the separate finite-inventory study.

AuthorsOpenReview ↗

Weaknesses 4–6, prior methods, semantics, and search

Weakness 4: Comparison with prior correlated samplers and the value of exact fidelity.

Thank you for asking us to make both comparisons precise. The mathematical advance is the exact individual-prefix optimum against arbitrary history-adapted admissible competitors and the necessary-and-sufficient characterization of every universal optimizer. One variance objective with positive weights on every nonroot node identifies the entire class. Section 3 (pp. 3–4), Section 6 (p. 10), and Appendix E (p. 26) distinguish this result from the classical systematic construction.

Another reviewer requested an identical-population adaptive comparison, which also strengthens the empirical baseline comparison you asked for. On the same 1,368 model–query rows, full PBD exceeds the token-order endpoint lattice by 0.104 points [0.009, 0.202], using a common controller and retained budget. These post-hoc nominal 95% intervals condition on boundary estimates. Appendix F.5 (p. 31) gives all five methods. The references compare finite-decoder contracts; complete online reproductions of Arithmetic Sampling and QuasiMoTTo remain outside the executed comparison.

The equal-budget example addresses why fidelity can matter. For P(A0,A1,B0,B1)=(1/4,1/2,1/16,3/16) and success {A0,B0}, two lanes expose their first tokens and one is retained. A consumer using base conditionals prefers A. At the same three-transition budget, success is 1/4 under endpoint coupling and 1/3 under PBD. Explicit endpoint recalibration obtains 3/8 under a different interface. Section 2 (p. 3) and Appendix F.1 (p. 27) establish the decision consequence without treating small average distortion as a measured real-task loss.

Weakness 5: Prefix occupancy does not guarantee semantic diversity.

We agree with the distinction and retain Proposition 2. To test whether the benefit survives a multiple-answer extension, we newly scored a canonical phrase and two natural paraphrases per intent, including EOS, and evaluated their union. Full PBD improves all six model–dataset means: 1.06 points on average, adjusted 98.33% interval [0.99, 1.13]. PBD4 retains 99.3% of that gain. The calculation integrates joint allocations rather than summing singleton hits.

Canonical phrases carry 99.4% of normalized mass on average. The positive result therefore concerns a modest, naturally scored extension, not arbitrary semantic-union optimality. Section 5.2 (p. 9) and Appendix F.2 (p. 28) report the same-prompt canonical control and complete comparisons.

Weakness 6: Repeated pruning, reward-guided selection, and dynamic allocation.

Based on this concern, we added a frozen, gold-free Qwen2.5-Math-PRM-7B controller retaining four unfinished lanes at depth 64 and two at depth 192, with no-pruning and one-pruning controls. All 94,968 requests include controller cost; unpruned controls retain the verifier. Selection is reward-guided, with depths and budgets fixed before evaluation rather than dynamically optimized.

Under two prunings and the 9.31 s deadline, success is 89.03%/88.78%/88.59% for IID/PBD4/full PBD. The primary full-PBD minus IID effect is −0.44 points, adjusted interval [−1.52, 0.66]. Comparisons are paired within matched execution blocks despite the configuration mixture. This adds the requested broader setting; the interval spans both directions, and Theorem 5 remains a common-state completion guarantee.

Section 5.4 and Appendix F.4 (pp. 10 and 30) report every schedule. We respectfully ask you to reconsider the paper in light of the complete characterization, consistent semantic extension, direct paired baseline comparison, and measured shallow-coordination profile.

Thank you for your time and effort.

Thank you for your detailed review and for recognizing the optimizer characterization and the promise of shallow coordination. We have brought the most relevant results together here to make our replies easier to follow. This comment covers realistic generation, inference cost, and absolute effect size; the next addresses prior couplings, semantic coverage, and adaptive selection.

1. Full-vocabulary reasoning and measured inference cost (concerns 1 and 3).

We evaluated Qwen2.5-7B-Instruct on all 1,319 GSM8K test questions, with four randomizations, K=8, and a 1,024-token cap. The 31,656 requests include fixed-K trials and actual deadline-limited trials. The online implementation obtains next-token probabilities at occupied prefixes, allowing it to work directly with autoregressive generation without enumerating complete output sequences.

MethodFixed-K median latencyFixed-K p95 latencySuccess by 9.31 s
IID6.39 s10.86 s96.38%
PBD46.40 s10.75 s96.38%
Full PBD6.74 s11.58 s96.10%

We set the deadline using training-only timing. An answer counts as successful if it is correct under the frozen final-line parser, has finished or reached the cap, and is available before the deadline. Methods share execution, precision, cache management, compaction, and instrumentation within matched blocks. We average randomizations within each question before paired question-level resampling. These choices keep the comparison consistent across methods and account for the complete request.

PBD4's median overhead is approximately 0.2%, calculated from unrounded timings. Its deadline-success difference from IID is 0.00 percentage points (pp), with adjusted 98.33% CI [−0.53, 0.55]. The success comparison does not establish an accuracy advantage, and peak-memory scaling and production throughput were not measured (Section 5.3; Appendix F.3). The practical finding is that shallow coordination runs at nearly IID median latency in this full-vocabulary reasoning workload.

PBD4 coordinates the first four global transitions and then uses fresh IID draws, preserving the per-lane conditional guarantee throughout. Exact prefixes cannot merge once they diverge, and a singleton group has no within-group allocation left to balance. The shallow variant therefore offers a concrete way to concentrate coordination early while keeping the conditional interface valid for the entire continuation.

2. Absolute effect size and the coverage price of the stronger guarantee (concern 2).

The canonical-label gain is 1.116 pp, recovering 99.5% of approximately 1.121 pp of endpoint headroom. The percentage describes the share of available improvement recovered. In this setting, PBD preserves almost all of the endpoint reference's coverage gain while retaining the stronger conditional guarantee.

The multiple-phrase study also shows consistency across models. With a canonical phrase and two natural paraphrases per intent, the full-PBD minus IID gains are:

ModelBANKING77 gain (pp)CLINC gain (pp)
Phi-3.5-mini+1.18+1.47
Qwen2.5-3B+1.09+1.11
Qwen2.5-7B+0.84+0.65

The mean across the six equally weighted settings is 1.06 pp, with multiplicity-adjusted 98.33% CI [0.99, 1.13]. Absolute semantic hit probabilities are 69.67% for IID, 70.72% for PBD4, and 70.73% for full PBD. PBD4 retains 99.3% of full PBD's aggregate improvement (Section 5.2; Appendix F.2).

All methods use the same model posteriors and query identities. The gain therefore comes from how the samples are coupled, with the underlying model probabilities held fixed. We find this encouraging: the coverage gain is consistent across six settings, and shallow balancing retains almost all of it.

The two studies answer complementary design questions. The finite-decoder study measures coverage gains from coupling; the online study measures actual generation cost and deadline success. We can therefore point to both a measured coverage gain in the finite-decoder setting and a working implementation for full-vocabulary generation.

3. Matched comparisons with endpoint coupling (concern 4).

In the matched adaptive comparison, every method uses the same 1,368 model–query rows, representing 456 distinct inputs. Temperature is 1 and K=8. After observing two transitions, the same target-free controller retains four lanes for continuation.

MethodTarget-free pass (%)
IID67.837
PBD468.879
Full PBD68.880
Token-order endpoint lattice68.776
Label-order endpoint lattice68.758

Full PBD exceeds the token-order reference by 0.104 pp [0.009, 0.202] and the label-order reference by 0.122 pp [0.020, 0.225]. These are post-hoc nominal 95% paired intervals, conditional on the stored boundary estimates. We resample queries within intents and preserve pairing across models and methods. With the same inputs, controller, and retained budget, PBD preserves the base conditionals and achieves higher measured success than both references in this finite-decoder setting.

The baselines here are finite-decoder endpoint references; complete online Arithmetic Sampling and QuasiMoTTo implementations were not evaluated. The comparison concerns utility at a common retained-lane budget, rather than matched runtime (Section 5.1; Appendix F.5).

Why the conditional interface can matter. The controlled example in Section 2 and Appendix F.1 holds the observed-history distribution and three-transition budget fixed. Two lanes reveal their first tokens and one is continued. The unchanged consumer prefers A, whose base success probability is 1/3, to B, whose probability is 1/4.

Coupling and consumerSuccess probability
Endpoint lattice, unchanged consumer1/4
PBD, unchanged consumer1/3
Endpoint lattice, recalibrated consumer3/8

On a mixed endpoint history, the A lane's actual success probability is zero; PBD preserves its base conditional after inspection. Recalibrating the endpoint consumer is a legitimate alternative, as the third row shows. The real-query comparison above separately measures success under the common controller. The example makes the benefit concrete: under PBD, a consumer that keeps using the original per-lane probabilities can continue to rely on them after inspecting the batch.

4. Several successful strings and semantic coverage (concern 5).

The multiple-phrase evaluation uses 7,610 distinct inputs across three fixed models, giving 22,830 model–query rows. We score the phrases naturally, including EOS, and calculate success on their union from joint sibling allocations. We resample queries within intents and share the resampling across methods and models, keeping repeated evaluations of each query together. This gives a controlled comparison of success when several phrases are accepted.

Canonical phrases retain 99.4% of normalized mass, and the same-prompt canonical-only control gives essentially the same gain. Proposition 2 keeps the distinction between individual-prefix optimality and arbitrary semantic-union optimality explicit (Section 5.2; Appendix F.2). Within this controlled extension, the positive gain survives the tested change to several acceptable phrases.

5. Repeated reward-guided selection (concern 6).

The 94,968-request study includes no-, one-, and two-pruning schedules with a frozen, gold-free Qwen2.5-Math-PRM-7B controller. The two-pruning schedule retains four unfinished lanes at depth 64 and two at depth 192. Depths and budgets are fixed in advance; controller cost is included, and unpruned controls keep the verifier resident.

At the 9.31 s deadline, two-pruning success is 89.03% / 88.78% / 88.59% for IID / PBD4 / full PBD. The full-PBD minus IID difference is −0.44 pp, adjusted 98.33% CI [−1.52, 0.66]. This does not establish an improvement for that policy (Section 5.4; Appendix F.4). Theorem 5 concerns continuation from the same once-selected state. The study directly addresses your request to test repeated reward-guided selection, with the controller's cost included.

The central theoretical result is a complete solution under the conditional requirement: Theorems 1–2 establish simultaneous individual-prefix optimality against arbitrary history-adapted admissible competitors and characterize every universal optimizer through local balancing. The paper brings together that exact design rule, positive controlled coverage and selective-continuation results, and a measured online implementation.

Thank you again for reviewing our work! We hope these replies have addressed your questions and clarified the contribution. We would appreciate it if you could revisit our responses and reconsider your evaluation score in light of these clarifications and results.

Reviewer_8GteOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper examines correlated sampling of multi-lanes concurrent completions in an autoregressive setting. The authors discuss that existing sampling techniques leak information about shared randomness to other lanes and can introduce bias in the future continual generation after inspecting partial generation. They introduce a stricter approach mandating each lane's next token follows the model's distribution provided the full public history. The proposed method addresses this issue by performing systematic resampling within groups of lanes that share an identical prefix. Key contributions include i) Universal Optimality theorem that shows PBD minimizes duplicate path allocation across all possible prefixes without requiring prior knowledge of target output, ii) The authors prove that an algorithm qualifies as a universal prefix optimizer if and only if it rounds branch counts to their nearest integer and iii) Structural results such as balancing deeper token steps monotonically improves output coverage and exposing extra intermediate steps can reduce achievable coverage. They test this across 3 models and 2 datasets. The PBD output had an increase in coverage by 1.1 pp and balancing only four levels kept 98.7% of the gain.

Critical strengths

The strengths of the paper include:

i) The identification of the hidden failure mode in multi-lane autoregressive decoding. While existing correlated samplers preserve the output probabilities, inspecting intermediate generation across lanes leaks shared background randomness and distorts the future next token probabilities.

ii) The strong and complete theoretical framework along with the structural theorems. They also explicitly prove the boundaries of their guarantees and where it does not extend.

Critical weaknesses

i) The post inspection probability distortion of standard samplers was extremely small. While the theory is sound, the experiments do not demonstrate where choosing PDB over standard samplers changes real world outcomes.

ii) The evaluation covers only short intent labels with pre-computed probabilities. In open-ended long form generation, lanes would diverge quickly and prefix groups should collapse to single lanes. PBD also requires real time prefix grouping and cross lane GPU synchronization at every token step introduces latency and overhead which might not be preferred.

Questions for authors

Can you demonstrate a synthetic or real world scenario where the post-inspection bias degrades downstream performance?

4 comments
AuthorsOpenReview ↗

Weakness 1 and Question 1, decision impact

Thank you for recognizing the conditional-validity distinction, the theoretical framework, and the explicit boundaries of the guarantees. We address your two weaknesses in order, combining your first weakness with your question because both ask for a consequential decision example.

Weakness 1 and Question 1: Can post-inspection distortion reduce downstream performance?

Thank you for asking for a decision-level consequence rather than only a distributional discrepancy. Yes: for a consumer that continues to use the decoder's original conditionals, an exact example gives success 1/4 under endpoint coupling versus 1/3 under PBD, with the same observation distribution and computation budget.

Let P(A0,A1,B0,B1)=(1/4,1/2,1/16,3/16), with success event {A0,B0}. Two lanes reveal their first tokens, and a controller retains one for its final token. The base success probabilities are 1/3 from A and 1/4 from B, so the controller chooses an A lane whenever available. Each policy spends exactly three token transitions.

For the endpoint lattice with coordinates S and (S+1/2) mod 1, where S is uniform, the histories AA, AB, and BA have probabilities 1/2, 1/4, and 1/4, exactly as under PBD. On a mixed endpoint history, however, the A lane's actual success probability is zero. On AA it is 1/2. The unchanged endpoint consumer therefore succeeds with probability (1/2)(1/2)=1/4. PBD preserves the retained A lane's conditional success probability of 1/3 after every history.

Coupling and consumerSuccess
Endpoint lattice, unchanged consumer1/4
PBD, unchanged consumer1/3
Endpoint lattice, recalibrated consumer3/8

The third row makes the alternative explicit: an endpoint-aware consumer can recalibrate and choose B on mixed histories. The design choice is therefore between preserving the reusable base-conditional interface and reconstructing the conditional law induced by the endpoint coupling. PBD gives the exact individual-prefix occupancy optimum under the former contract.

This directly answers your request for a synthetic or real scenario. The measured mean distortion on short labels remains small; the example establishes a consequential case rather than its prevalence across real tasks. Section 2 (p. 3) now explains the consumer before the main theorem, and Appendix F.1, Table 19 (p. 27), gives the complete calculation. The motivation is thus supported by a controlled decision consequence, with the alternative interface explicitly accounted for.

AuthorsOpenReview ↗

Weakness 2, online generation and prefix divergence

Weakness 2: Short-label evaluation, prefix divergence, and coordination overhead.

We agree that this concern calls for actual autoregressive generation rather than inference from precomputed intent scores. Based on your feedback, we added a full-vocabulary GSM8K study using Qwen2.5-7B-Instruct on all 1,319 test questions, four randomizations, K=8, and a 1,024-token cap. The 31,656 requests cover fixed-K and actual deadline-limited comparisons.

MethodFixed-K median latencySuccess by the 9.31 s deadline
IID6.39 s96.38%
PBD46.40 s96.38%
Full PBD6.74 s96.10%

PBD4's median is approximately 0.2% above IID, calculated from unrounded timings, and both have the same observed deadline-success estimate. The primary PBD4 minus IID difference is 0.00 percentage points, adjusted 98.33% interval [−0.53, 0.55]. This provides a concrete shallow-coordination cost profile; the interval does not establish superiority or formal equivalence. Success requires a correct completed or capped answer satisfying the frozen final-line parser before the deadline, which was fixed from training-only timing.

Your prefix-divergence observation also helps explain the value of shallow coordination. Once exact prefixes differ, those groups cannot merge; a singleton group has no within-group allocation to balance. PBD4 coordinates only the first four global transitions and uses IID thereafter, without restarting the cutoff when groups split. It retains the conditional contract without coordinating the entire continuation. The depth-four choice is evaluated here, not asserted to be universally sufficient.

A related request from another reviewer led us to allow several correct phrases per intent. That study also bears on your cost concern: PBD4 retains 99.3% of full PBD's gain, and full PBD's aggregate improvement remains positive after multiplicity adjustment. This supplies evidence about what shallow balancing retains in the finite inventory, alongside the separate online timing measurement.

Methods share model, cache, compaction, and instrumentation within matched execution blocks. The timings therefore measure the implemented pipeline, rather than isolated grouping cost against a separately optimized asynchronous baseline.

Where the revision answers this concern. Section 5.3 (pp. 9–10) and Appendix F.3, Tables 22–23 (p. 29), report timings, deadline success, and paired uncertainty; Supplement S.1 explains the shared execution design. Together with the decision example, these additions connect the conditional guarantee to an explicit consumer and a promising shallow implementation. We hope they strengthen your assessment of the contribution.

Thanks again for your time and effort.

Thank you for the detailed response and additional experiments. The decision level example addresses my concern about the practical consequences of post inspection bias and the GSM8K evaluation provides useful evidence of PBD4's feasibility with minimal latency overhead. Some questions about generalizability across models and longer form generation remain. Nevertheless, the theoretical contribution is there and the revisions sufficiently address my primary concerns. I maintain my Weak Accept recommendation.

Thank you for your thoughtful follow-up and for maintaining your Weak Accept recommendation. We are glad that the decision-level example and the online GSM8K evaluation addressed your primary concerns. Your questions helped us explain more clearly when post-inspection conditional fidelity matters and how shallow coordination works in practice.

We also appreciate your remaining questions about other models and longer outputs. The finite-decoder experiments cover three checkpoints and two datasets, while the online evaluation covers Qwen2.5-7B-Instruct on GSM8K. The theoretical guarantee applies to fixed finite-horizon autoregressive decoders. PBD4 coordinates the first four global transitions and then uses fresh IID draws, preserving each lane's conditional interface throughout the continuation. This gives a clear guarantee for the sampling process; the effect of early coverage on final answer quality and runtime for other models and longer outputs remains a question for further evaluation.

Thank you again for the time and care you have put into reviewing our work.

Comments on the paper

2 comments
AuthorsOpenReview ↗

Exact characterization and consistent gains

We thank the reviewers for recognizing the theoretical contribution and the promise of shallow coordination. PBD gives an exact individual-prefix occupancy optimum on a fixed decoder tree over all history-adapted couplings satisfying the public-history conditional contract, and characterizes the entire class of universal optimizers. This includes competitors using arbitrary off-path history and cross-group dependence, not merely a fixed collection of sampling heuristics.

The strongest new evidence. With three naturally scored phrases per intent, full PBD improves semantic-class hit probability in all six model–dataset cells. The equal-cell gain is 1.06 percentage points, with a multiplicity-adjusted 98.33% interval [0.99, 1.13]. PBD4 retains 99.3% of this gain. Separately, in full-vocabulary GSM8K generation, PBD4's fixed-K median latency is 6.40 s versus IID's 6.39 s, approximately 0.2% higher when calculated before rounding. These complementary measurements identify a promising practical choice: shallow coordination preserves nearly all the measured finite-inventory benefit while operating at nearly IID median latency in the online study.

Shared concern: What is mathematically new? We appreciate the requests to distinguish the contribution from classical systematic sampling. Theorem 1 establishes simultaneous convex-order optimality for every individual prefix count. Theorem 2 proves both sufficiency and necessity: local floor/ceiling child counts characterize every universal optimizer. Equivalently, one variance objective with positive weight on every nonroot node identifies the same class. The systematic grid realizes this optimum; the contribution is the dynamic optimum and its complete characterization. Section 3 (pp. 3–4) gives these results, and Appendix A supplies the proofs.

Shared concern: Why preserve conditionals after inspection? We agree that the intended consumer should be concrete. A controller may inspect the whole partial batch and allocate continuation resources using the decoder's original prefix probabilities. PBD preserves that interface after inspection; endpoint marginals alone need not. Section 2 (p. 3) and Appendix F.1 (p. 27) now give an equal-budget decision example, including an explicitly recalibrated endpoint alternative. This makes the distinction operational rather than purely definitional.

How the added evidence strengthens the paper. The revision directly addresses the requests for multiple successful strings, online generation, repeated reward-guided pruning, and identical-population comparisons. Full PBD provides the exact prefix-count optimum, while PBD4 offers a shallow, contract-preserving implementation with a measured cost–benefit profile. Our reviewer-specific replies answer each weakness and question in its original order.

AuthorsOpenReview ↗

Requested evaluations and manuscript changes

Thank you for asking us to connect the controlled finite-decoder results to practical generation and adaptive consumption. We have added the requested evaluations so that the conditional interface, empirical benefit, and computational cost can be assessed together.

Online generation and matched time. We evaluated Qwen2.5-7B-Instruct on all 1,319 GSM8K test questions, with four randomizations, K=8, and a 1,024-token cap: 31,656 requests across three methods and two budget conditions.

MethodFixed-K median latencySuccess by the 9.31 s deadline
IID6.39 s96.38%
PBD46.40 s96.38%
Full PBD6.74 s96.10%

PBD4 has nearly IID median latency and the same observed deadline-success estimate. Its paired difference is 0.00 percentage points, adjusted 98.33% interval [−0.53, 0.55]. This supports the measured shallow-coordination profile. The deadline was fixed using training-only timing; success requires a correct completed or capped answer satisfying the frozen final-line parser before that deadline. Section 5.3 (pp. 9–10) and Appendix F.3 (p. 29) explain this complete-request measurement and its shared instrumentation.

Identical-population comparison. The matched comparison requested by one reviewer also addresses the broader question of utility relative to endpoint coupling. On the same 1,368 model–query rows, representing 456 distinct inputs, full PBD exceeds the token-order endpoint lattice by 0.104 points [0.009, 0.202] and the label-order lattice by 0.122 points [0.020, 0.225]. Section 5.1 (pp. 6–9) and Appendix F.5 (p. 31) report these post-hoc nominal 95% paired comparisons, conditional on boundary estimates. They compare a common controller and retained budget, not equal runtime.

Repeated reward-guided pruning. We also added a frozen, gold-free Qwen2.5-Math-PRM-7B controller, retaining four unfinished lanes at depth 64 and two at depth 192. The 94,968-request study includes controller cost and unpruned controls with the verifier resident. The primary timed full-PBD minus IID effect is −0.44 points, adjusted interval [−1.52, 0.66]. This evaluates the requested broader controller setting; its interval spans both directions. Section 5.4 (p. 10) and Appendix F.4 (p. 30) distinguish this policy-level measurement from Theorem 5's common-state continuation guarantee. Comparisons are paired within matched execution blocks, with the configuration mixture documented in the supplement.

What changed and what remained unchanged. The public-history contract and Theorems 1–6 remain unchanged. Supplement S.4 records the historical adaptive suffix-dispatch correction: balanced observation had incorrectly been followed by IID completion. Static results and nonnegative-depth variants were unaffected; the adaptive tables use corrected full-depth values.

The revision now connects the exact characterization to consistent multi-phrase gains, a direct paired adaptive comparison, and a measured shallow-coordination tradeoff. We respectfully ask reviewers to reconsider their assessments in light of this strengthened evidence and the clearer answers to their individual concerns.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

Related papers

Loading the map…

Discussion (0)

Sign in to comment.