- Rating
- 3
- Confidence
- 3
- Informativeness
- 2
- Presentation
- 3
- Soundness
- 3
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Paper summary
The paper introduces a new conditional diffusion framework, PTSDiff, for multiple different physiological time-series restoration. The paper claims that the physiological time-series data contain wide-sense cyclostationarity property, and leveraging this information for training improves the performance. In particular, the model uses shift-covariant representation to satisfy that property and uses phase information as additional conditioning input. The results show that PTSDiff achieves the best performance in most of the datasets on three different metrics.
Critical strengths
The paper is well-written and easy to follow. The conditional diffusion on shift-covariant wavelet representation model design is clean and novel. The experiments provide a comprehensive evaluation and show superior performance compared with other baselines.
Critical weaknesses
Unclear contribution of phase conditioning: the two main novelties of PTSDiff are “training diffusion on a shift-covariant wavelet representation” and “using dense per-sample phase conditioning inferred from the corrupted input”. However, the phase conditioning contribution is unclear.
- Only ECG phase encoder is warm-started toward phase targets. Other three modalities directly learn the phase encoder from the corrupted data y. Therefore, it is unclear if the phase encoder really learns the phase information or simply acts as an additional feature encoder for the denoiser. Could the authors verify what the learned channels represent, e.g., by comparing the predicted phase with detector-derived phase?
- The phase-shuffle experiment in Figure 2 is to support the claim that “phase conditioning helps more when cycle structure is stronger”. However, permuting any informative per-sample conditioning would reduce performance, so the drop shows that the model relies on the branch, not that the branch encodes phase or how much it helps. The retrained ablation in Table 17 is a clearer measure of the benefit, and it shows a much smaller effect than the shuffle drop. In addition, the y-axis of Figure 2(b) (the ΔSNR margin over the best baseline) also depends on the strength of each modality’s baseline, and the correlation rests on only four points. In my opinion, plotting the Table 17 benefit on using phase conditioning against the cyclostationarity index in Table 18 would more directly support the claim.
Questions for authors
Clarification requests:
- According to section 3.2, “the undecimated transform is a tight frame with A = B = J+1”. However, the provided code uses the unnormalized SWT from pywt, which should give us the frame bounds A = 2, B = 2^J = 16. The frame is therefore not tight and the constant in equation 11 needs to be corrected.
Suggestions for future work:
- PTSDiff uses SWT coefficients for diffusion training, and the benefits are clear that it is shift-covariant. However, it is redundant as mentioned in section 3.2. The valid coefficients form only an L-dimensional subspace of the 5L space. However, diffusion model adds and predicts noise on all 5L dimensions, and the noise in the remaining 4L directions is exactly predictable from x_t^F. Can the author explain why this redundancy is not an issue? For example, if the predicted clean coefficients \hat{x}_0^F were projected onto the valid coefficients at every reverse step, i.e. \hat{x}_0^F <- swt(iswt(\hat{x}_0^F)), which would set the 4L components to 0, would it improve or hurt the model? I think the effect of the redundant space on diffusion is worth analyzing.
- Inference computation: Table 21 compares the model parameter, NFE, and wall-clock time with DeScoD-ECG and TFCDiff, but only on ECG. The deterministic baselines (DDAE, TCDAE, FCN, EEGIFNet) require a single forward pass (NFE = 1), and the stochastic baselines on the other modalities (SDEMG, EEGDfus) appear to use a single sample rather than MC-K or AV-K averaging. It would be better to also include the NFE and inference time for all baselines, and either apply averaging to the stochastic baselines or report PTSDiff without averaging. It is fine to have larger inference computation for better performance, but I believe this trade-off is worth mentioning.
- Training computation: It would be better to include the training time as well to help readers gauge the computational requirements.
3 comments
Response to Reviewer dN14 - Part 2
Redundancy in SWT-Domain Diffusion (Suggested Future Work 1)
We thank the reviewer for this interesting suggestion. We agree that the redundant SWT representation introduces additional dimensions, including noise components outside the valid coefficient subspace, potentially increasing computational cost. However, this does not prevent valid time-domain reconstruction, as the synthesis operator maps predicted coefficients back to the original signal space. Projecting the predicted clean coefficients onto the valid SWT subspace at each reverse step would enforce coefficient consistency, but could also alter the learned reverse dynamics. Whether this improves restoration quality requires empirical investigation, and we consider it an interesting direction for future work.
Meanwhile, we provide additional ablations comparing SWT against alternative representations (Appendix D.12, Table 24), supporting its empirical effectiveness despite the redundancy.
Inference Computation (Suggested Future Work 2)
Thank you for the suggestion. We agree that the comparison should be complete and the trade-off stated. One clarification first: the SDEMG and EEGDfus rows of Table 1 were already averages over ten trajectories, the same protocol as DeScoD-10 and TFCDiff-10, but their labels and our protocol description did not say so. We have renamed them SDEMG-10 and EEGDfus-10 and corrected the text for more clarity. All stochastic baselines are therefore compared under the same averaging as PTSDiff.
Table 25 (previously Table 21, ECG only) now covers every model of Table 1 in all four modalities, with NFE, parameters and wall-clock time per segment on a single NVIDIA RTX 4090 at batch size 32. As you suggested, it also reports PTSDiff without averaging (MC-1). For completeness we add one antithetic pair (AV-2) for PTSDiff and for every diffusion baseline. All values are means over three training seeds.
With one antithetic pair, PTSDiff exceeds every baseline in all four modalities, at a lower wall-clock time than each averaged diffusion baseline. The single-pass models remain far cheaper (0.1 to 0.4 ms against 19 to 278 ms) in terms of latency; the extra cost buys 3.3 to 4.2 dB on PPG, ECG and EMG but only 0.3 dB on EEG. We now state this inference-time to performance trade-off next to Table 25 in Appendix Section D.14.
Training Computation (Suggested Future Work 3)
Thank you for the suggestion. The revision now reports the training cost of PTSDiff and each baseline in Table 6 (Appendix C.2), measured on a single NVIDIA RTX 4090. The training part for our model is reproduced here:
| Modality | Dataset | Params [M] | Segments | s/epoch | Epochs | Total [h] |
|---|---|---|---|---|---|---|
| ECG | PTB-XL | 3.44 | 17,441 | 40 | 500 | 5.8 |
| PPG | PPG-DaLiA | 3.44 | 21,284 | 35 | 300 | 2.9 |
| EEG | EEGdenoiseNet | 9.88 | 29,920 | 57 | 420 | 6.7 |
| EMG | NinaPro DB2 | 3.44 | 159,960 | 1411 | 60 | 23.5 |
A single training run takes between 2.9 h (PPG) and 23.5 h (EMG) on the GPU. Training all four models once takes about 39 GPU-hours in total (the sum of the last column). EMG dominates because of its longer windows (L = 10,000) and a training set five to nine times larger than the others. Each total is the median duration of three timed epochs, measured after one warm-up epoch, multiplied by the configured number of epochs. Totals exclude per-epoch validation; the ECG total includes the phase-encoder warm-start (0.3 h).
Thank you for the authors' response. Most of my concerns has been resolved, including the SWT frame bound, inference computation, training computation, and the phase-shuffling experiment.
Regarding the "Redundancy in SWT-Domain Diffusion", the authors provide a new ablation on using different transformed representation to show the advantage of SWT-domain diffusion, and the results are clear. The authors list the redundancy analysis as future work.
Regarding the "Physiological Phase Conditioning", the new matched-capacity ablation on ECG supports the benefit of phase-informed initialization. For the other three modalities, the authors explain the difficulty of extending explicit phase supervision and revise the claim to "phase-inspired learned temporal conditioning". Although this makes the paper's claim weaker, it is now more honest and better supported by the evidence.
In conclusion, the authors' response resolves most of my concerns, with the remaining questions either deferred to future work or addressed by narrowing the claims. I am happy to remain my score of 3 (Weak acceptance).
Response to Reviewer dN14 - Part 1
We thank the reviewer for their thoughtful feedback and suggestions. Below, we address each point individually.
Clarification of Physiological Phase Conditioning (Weakness 1)
We agree that, without explicit phase supervision, the learned encoder is not guaranteed to recover interpretable physiological phase.
For ECG, where a reliable analytical peak detector is available, we initialize the encoder with detector-derived phase targets before jointly optimizing it for restoration. We now provide an analysis of phase-estimation errors throughout training Appendix D.15, Figure 12) to assess how closely the learned representation remains aligned with physiological phase. Furthermore, a new matched-capacity ablation (Appendix D.8, Table 20) shows that phase-informed initialization improves restoration compared with training the same encoder from scratch, demonstrating the benefit of incorporating explicit physiological phase information beyond additional model capacity.
For PPG, EMG, and EEG, where no explicit phase supervision is used, we acknowledge that the learned channels may represent more general temporal features rather than physiological phase. We therefore revise the title and manuscript to distinguish phase-informed initialization for ECG from phase-inspired learned temporal conditioning for the other modalities.
Extending explicit phase supervision to these modalities is not straightforward and remains future work, because none of them offers a reliable analytical phase target comparable to the ECG R-peak. PPG has a well-defined cardiac cycle, but beat detectors degrade under the motion artifacts that dominate wrist recordings (Charlton et al., 2022), and borrowing targets from a synchronous ECG would require a second sensor and a pulse arrival delay that itself varies from beat to beat. Surface EMG is the superposition of many motor units firing at different rates, so it has no single cycle to supervise, and its firing structure is recoverable only by decomposing multi-channel recordings (Farina et al., 2004; Holobar & Zazula, 2007), which our single-channel setting does not provide. EEG oscillations are bursty, non-sinusoidal and band-specific, so a phase exists only within a band and only while an oscillation is present (Cole & Voytek, 2017; Donoghue et al., 2020), which rules out a single dense target of the kind in Eq. (7). We have made this clear in the revised version and added to the future work section.
References
Phase-Shuffling Experiment and Revised Figure 2 (Weakness 2)
We agree on all points. The shuffle measures how much the trained model relies on the branch, not what the branch encodes or how much it helps, and the margin over the best baseline also reflects baseline strength. We have made the change you suggested: Figure 2(b) now plots the gain from phase conditioning in the retrained ablation (full model minus no-phase model, Table 18) against the cyclostationarity proxy ΠAC (Table 21, modality mean). The old panel is removed, and the text now presents the shuffle only as a measure of reliance. The panel still has only four modalities, so we use it to show the trend that modalities with stronger cycle structure gain more, not as conclusive statistical evidence. Additional supporting evidence for the trend is the synthetic sweep, with 21 controlled conditions (Figure 3, r = 0.85).
Clarification of SWT Frame Bounds and Eq. (11)
Regarding Clarification Request 1, we thank the reviewer for checking this against the code. You are correct: we use the unnormalized SWT, whose frame bounds are A=2 and B=2J=16, so the frame is not tight and our statement A=B=J+1 was wrong. We apologize for the oversight and appreciate the comment.
We have corrected Section 3.2 and the text following Eq. 11. The bound keeps its form, but its constant is now A−1/2=2−1/2 instead of (J+1)−1/2, as justified by the operator norm of the synthesis operator used in our implementation (Appendix C.2). A new paragraph in Appendix C.2 gives the filters, the synthesis operator, the frame bounds and a short justification of this norm. The implementation and all reported experimental results are unchanged, since the correction only affects the theoretical analysis motivating the auxiliary losses.