acceptodds
Withdrawn from ICLR 2027

When Control Knobs Mislead: Diagnosing and Calibrating Reference Control Under Incremental Commitment

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Inference-time reference controls can change generated images, videos, and motions, yet users may still be unable to select the intended intermediate effect. We study this failure of effect selection under incremental commitment, where tokens or temporal blocks become fixed before generation ends. A duration setting can then cover very different target commitments, concentrating most response change within a short parameter interval. Our goal is to determine when such a control can be corrected without retraining and when its sampling or measurement assumptions need revision. Because learned samplers combine exposure timing with contextual prediction, we isolate timing in an independent-token model. With fixed commitment times and a hard duration gate, the normalized expected response equals the fraction committed before reference release. Thus timing alone can concentrate a response without establishing that intermediate effects are unavailable, motivating inverse-response calibration. We derive a conditional transfer bound to explain why fitting that inverse on development tasks cannot guarantee accurate requests on new tasks and seeds. We also derive an endpoint-perturbation bound because normalizing effects by a small zero-to-maximum-control gain can make the evaluation itself unstable. These results guide commitment-order and overwrite ablations and frozen standard isotonic calibration across seven controller recipes. We compare five generators and test calibration on three masked models using twelve held-out tasks and three seeds per model. Confidence-duration hit rates rise from 16.0% to 40.1% for Meissonic and from 20.1% to 44.1% for Show-o. MoMask shows no mean error reduction, even on valid confidence-duration requests. Its unmatched decoder dependencies identify a conditional risk for motion architectures: controlling partial latent codes need not secure a reliable decoded endpoint. Reliable effect selection therefore requires both a transferable parameter map and a stable effect scale; response width alone establishes neither.

Primary area:
generative models
Keywords:
Inference-time generative control, Incremental commitment, Reference-duration control, Response concentration, Inverse-response calibration, Calibration transfer, Endpoint perturbation, Masked image and motion generation.

Reviews

Among:
Shape:
1234this paper, Bottom 2%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.33 over 3 reviews, above 2% of the others.
Reviewer_wzvGOpenReview ↗
Rating
1
Confidence
3
Informativeness
3
Presentation
2
Soundness
2
Read review
Paper summary

This paper studies the mismatch between nominal control parameters and their actual effects in generative models, with a focus on reference control under incremental commitment. It analyzes how commitment timing affects control responses and proposes a post-hoc calibration approach based on isotonic regression. Experiments examine several image, motion, and video generators, showing improved calibration for some models while also identifying cases where calibration is less effective.

Critical strengths
  1. The paper addresses a practical and meaningful problem: a linear change in a control parameter does not necessarily produce a proportional change in the generated output. The analysis of incremental commitment provides a useful perspective on this issue.
  2. The empirical study covers multiple generators and control configurations. The authors also report and analyze negative results, which helps clarify the limitations of the proposed calibration approach.
Critical weaknesses
  1. Although the paper provides a useful analysis of reference control under incremental commitment, its calibration approach shares a similar motivation with prior work such as FreeSliders. The distinction from existing nonlinear control reparameterization methods could be clarified. Moreover, the theoretical analysis relies on simplified assumptions, and a direct quantitative comparison between its predictions and the responses of real generators is not provided. The main figures could also better emphasize the key findings beyond conceptual illustrations.
  2. The abstract discusses five generators, but systematic quantitative calibration experiments are conducted on only three. A fitted linear calibration baseline would help clarify the benefit of isotonic regression. In addition, the submitted PDF does not support text selection or searching, and the repeatedly referenced appendices are neither included in the PDF nor available as supplementary files, making several experimental and theoretical details difficult to verify.
Questions for authors

Please refer to the weaknesses above. Could the authors clarify the novelty of their calibration approach relative to FreeSliders, quantitatively validate Eq. (4), and include a fitted linear calibration baseline? Please also provide the missing appendices and a searchable PDF.

2 comments

Thank you for recognizing the practical control problem and the value of reporting negative results. We have clarified the relation to FreeSliders and the scope of each experiment. FreeSliders detects and remaps concept-slider traversal ranges; our study examines reference-duration controls whose response depends on the order in which sampler states become fixed. We use standard isotonic regression as the calibration procedure and focus on commitment-order effects, the shared effect scale, and held-out transfer. We do not claim a new isotonic algorithm or superiority over FreeSliders.

The independent-token derivation is exact under its stated fixed-time assumptions, and Monte Carlo validates that identity for the synthetic sampler. The real-model experiments intervene on commitment order and measure resulting response widths. They support the claim that order can change response concentration, but they do not quantitatively fit Equation (4) to neural outputs. We have made this distinction explicit in the revised manuscript.

Five generators appear in the comparative control study; prospective calibration is evaluated on three masked models. We now state that split directly in the abstract and experiment description. The fitted affine calibration baseline has not been evaluated. Our quantitative calibration claim is therefore limited to the comparison between frozen isotonic selection and native α=β\alpha=\beta selection; these results do not establish an isotonic advantage over a linear map.

The revised PDF now contains Appendices A–H and searchable text. The first-stage omission was ours, and we recognize that the missing material prevented verification in the version you received.

Thank you for the response and the revised manuscript. However, I have serious concerns about the unusually extensive revisions. The changes are not limited to correcting the missing appendices or improving presentation. Large portions of the abstract, introduction, method, experimental discussion, and even the limitations section have been rewritten, with substantial changes to figures and tables as well. The revisions appear to affect nearly every major section of the paper, making it difficult to regard the revised manuscript as a straightforward clarification of the original submission.

More importantly, my main technical concerns remain unresolved. The authors acknowledge that Eq. (4) has not been quantitatively validated on real generators and that a fitted linear calibration baseline has not been evaluated. The response primarily narrows or clarifies the claims rather than providing the evidence needed to address these concerns.

I also expect the authors to take full responsibility for the accuracy and quality of their submitted work, as stated in their AI Use Statement.

Reviewer_M4mQOpenReview ↗
Rating
2
Confidence
3
Informativeness
1
Presentation
3
Soundness
2
Read review
Paper summary

This work investigates the effect of reference-control parameters on the outputs of generative models. Given a generative editing task and a reference input, the authors study how introducing or removing reference information at different stages of generation influences the resulting output. The study covers multiple generative settings, including image tokens, motion tokens, and video blocks.

The central question is whether adjusting a control parameter between 0 and 1 produces the degree of change expected by the user. The contributions are twofold. First, the authors investigate how token commitment schedules influence response concentration, where most of the generated output's variation occurs within a narrow range of the control parameter. Second, they propose calibrating the control parameter by learning an inverse mapping between the requested effect and the measured response, allowing more predictable control over generation.

Critical strengths
  1. Thorough and well-structured investigation: The paper presents a systematic investigation of how control parameters influence generative outputs. It clearly distinguishes response concentration, calibration transfer, and endpoint stability, allowing the individual factors affecting controllability to be studied separately.

  2. Evaluation across different generative settings: The experiments cover different generative representations, including masked image tokens and motion tokens, with additional exploratory analysis of video-block generation. Particularly interesting are the experiments on motion generation, where calibration provides no meaningful improvement. This is an important observation, demonstrating that controlling part of a latent representation does not necessarily translate into equivalent control over the final decoded output.

  3. Systematic analysis of commitment policies: The paper investigates four primary commitment policies and extends the analysis to additional configurations. The experiments are systematically designed, and the figures effectively illustrate how different commitment schedules influence response concentration and calibration.

Critical weaknesses
  1. Insufficient motivation and positioning: The paper could better establish its position relative to existing work. While the related work section introduces several approaches to inference-time generative control, it does not sufficiently discuss their limitations or explain the specific research gap addressed by this study. Similarly, the introduction could better motivate why the relationship between control parameters, commitment schedules, and response concentration is important. Several key concepts are introduced without sufficient intuition, making the overall flow of the paper difficult to follow despite the formal definitions provided later.

  2. Limited qualitative visualization of response concentration: While the paper provides clear diagrams and quantitative analyses, additional qualitative examples could help readers better understand the effects of response concentration on generated outputs. In particular, visualizing how outputs change across closely spaced native control parameters, especially within narrow response intervals, would provide a more intuitive understanding of the phenomenon.  Figure 5 provides examples of generated outputs at different requested effects, but a direct visualization of native response concentration would complement the quantitative analysis.

  3. Missing appendix: The paper frequently refers to additional experiments, implementation details, and analyses presented in Appendices A–E. However, these appendices are not included in the provided manuscript PDF.

  4. Lack of clarity and structure in Sections 4 and 5: Sections 4 and 5 introduce several important concepts without sufficiently establishing their motivation or explaining how they connect to the central research question. Section 4, in particular, combines multiple ideas, including response concentration, common effect scales, inverse calibration, and calibration error, without clearly explaining the intuition behind each component or how they fit together. This makes the proposed calibration procedure difficult to follow. Similarly, Section 5 introduces the evaluation methodology and several metrics without first clearly establishing the specific questions the experiments aim to answer or what outcomes would demonstrate successful calibration. A more structured presentation that introduces the motivation, intuition, and expected outcomes before the mathematical formulations and evaluation protocols would significantly improve readability.

  5. Insufficient motivation and interpretation of mathematical formulations: Sections 3–5 introduce several mathematical formulations without sufficiently explaining their motivation or clarifying the relationships between them. While the individual equations appear mathematically consistent, the paper does not clearly distinguish between measurement definitions, theoretical derivations under simplifying assumptions, and calibration-error decompositions. In particular, Equations 1 and 2 introduce different normalizations of control response, but the distinction between their purposes and the motivation for the common effect scale could be explained more clearly. Similarly, Equations 3–4 establish a relationship between commitment timing and response concentration under a simplified independent-token model. However, the implications of these assumptions for real generative models could be discussed more explicitly. Finally, Equations 5–6 introduce calibration-error and endpoint-sensitivity bounds, but their implications for the proposed calibration procedure and subsequent experiments are not sufficiently developed. The main concern is not mathematical correctness, but rather that the paper does not clearly communicate what each formulation establishes, why it is necessary, and how it motivates the subsequent experiments.

Questions for authors
  1. Motivation and relationship between mathematical formulations: Please clarify the motivation behind the different mathematical formulations introduced in Sections 3–5? In particular, what is the conceptual distinction between the normalized response in Equation 1 and the common effect scale in Equation 2? Why are both necessary, and how do they contribute differently to the analysis of controllability? A more explicit explanation connecting these formulations to the subsequent calibration procedure would be helpful.

  2. Assumptions underlying the theoretical analysis: Equations 3–4 establish a relationship between commitment timing and response concentration under an independent-token model with fixed commitment times. How closely do these assumptions reflect the behaviour of the evaluated generative models, where token predictions are context-dependent and commitment schedules may change during generation? Please clarify which conclusions from the simplified analysis are expected to hold in practical settings and how the experiments validate these conclusions?

  3. Interpretation of the calibration-error bounds: Equations 5–6 provide bounds on calibration transfer error and the sensitivity of the normalized response to endpoint perturbations. Could the authors elaborate on how these bounds inform the calibration procedure or the interpretation of the experimental results? In particular, how do these theoretical observations help explain the differences in calibration performance between Meissonic, Show-o, and MoMask?

1 comment

Thank you for highlighting the value of separating response concentration, calibration transfer, and endpoint stability, as well as the negative MoMask result. We revised the presentation so that each equation is introduced by the question it answers.

Equation (1) normalizes a controller by its own endpoints and measures response shape: how much of the native α\alpha interval contains the central 80% of its endpoint-normalized change. Equation (2) uses the same confidence-duration anchor for each policy on a task and seed. It measures the requested decoded effect on a common reference-distance scale. The first makes widths comparable across policies; the second tests whether a selected parameter achieves the same requested effect. Calibration uses the second scale to map a requested β\beta to α\alpha.

Equations (3)–(4) derive an exact expected token-match response under independent candidate matches, fixed commitment times, and the specified overwrite gate. The resulting response is a commitment-time CDF. These assumptions isolate the timing contribution. In neural models, context, adaptive commitment, and decoding also affect the measured response, so our real-model evidence is an order intervention: target-first versus target-last substantially changes image-model response width. The synthetic Monte Carlo checks the toy identity; the neural experiment tests the direction of the timing effect, not a quantitative fit of Equation (4) to decoded outputs.

Equation (5) decomposes held-out request error into inverse residual, development-fit error, task shift, and seed variation. Freezing the map before evaluation makes the final two terms observable in held-out results. Equation (6) shows that endpoint-distance perturbations are amplified when anchor gain is small. This matches the observed contrast: image-model confidence calibration improves held-out hits, whereas MoMask has 8/36 nonpositive anchors and its 252 valid slots remain at 0.3821 versus 0.3823 mean bounded error before and after calibration. The bounds organize these measurements; they do not assign MoMask's errors to one decoder component.

We agree that a native-α\alpha visual sequence would help readers see the concentrated interval directly. The current revision clarifies the role of the native response curves and Figure 5's requested-effect examples, but it does not add a matched visual sequence across closely spaced α\alpha values. We do not treat Figure 5 as evidence for that visualization. The revised PDF includes the omitted appendices A–H.

Reviewer_igKiOpenReview ↗
Rating
1
Confidence
3
Informativeness
1
Presentation
1
Soundness
1
Read review
Paper summary

This work studies the calibration issue in reference control in generative models. Specifically, in masked generative models, the authors analyze how the timing and order in which tokens become fixed affect the response to reference control. This paper then introduces a toy model assuming independence of tokens, demonstrating how normalized expected response is determined by the distribution of the timings of the token fixation. The authors then propose a method to calibrate the control parameters using inverse-response function. Finally, they benchmark the methods and report improved target-hit rates after calibrating confidence duration control for Meissonic and Show-o, but MoMask did not demonstrate improvement.

Critical strengths

Please see the weaknesses section.

Critical weaknesses

The submitted manuscript suffers from critical clarity issues. The abstract on OpenReview doesn't match with the one in the submitted pdf. The writing is difficult to follow, while related works section is sparse. Most critically, Appendix A-H, that the authors often reference throughout the main text could not be found.

Questions for authors

I recommend that the authors substantially improve the presentation and resubmit the paper to a future conference.

1 comment

Thank you for identifying two serious submission errors: the OpenReview abstract differed from the PDF, and we omitted Appendices A–H. Both were our responsibility. The revised PDF now has the corrected abstract, includes Appendices A–H, and is searchable; we will use the same abstract text in the OpenReview field. We understand that these corrections cannot change the version you initially reviewed.

We ask that the soundness score be tied to a technical issue in the paper. The weaknesses listed in the review concern clarity, related-work coverage, the abstract mismatch, and the missing appendices. They identify no incorrect proposition, violated assumption, inconsistent statistic, or result contradicted by the evidence. Those presentation and submission failures warrant correction, which we have made; they do not specify why the analysis is unsound. If there is a particular mathematical or empirical flaw behind the soundness score of 1, please identify it so we can address it directly. Otherwise, we ask that the soundness assessment distinguish the documented presentation failures from technical validity.

Your summary accurately describes the timing analysis, the held-out calibration study, and the negative MoMask result. We therefore also ask for clarification of the informativeness score of 1: which central result or connection do you consider uninformative? A specific point would help us respond to the substance of that assessment.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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