acceptodds
Under review as a conference paper at ICLR 2027

Does an Agent Know How Far It Has Gone? Tracing Task Progress Representations During Long-Horizon Tool Use

Abstract

Long-horizon LLM agents must maintain an evolving task state that reflects what has been resolved and what remains to be done as new evidence arrives. We study this internal state of agents as task progress representation. Yet prior work has largely examined intermediate execution through explicit outputs or observable behaviors, leaving unclear whether such a representation exists and evolves during execution, a question requiring an external progress reference and controls for confounds such as task identity and interaction depth. Leveraging externally verifiable task constraints and matched comparisons, we identify residual directions that reflect verified task progress and thus provide evidence for an internal task progress representation, specifically at two execution points: (the first token after the latest observation) and (the first answer token after reasoning). We trace how this representation evolves through execution: when new tool observations yield larger verified progress gains, the internal progress signal advances further and is largely preserved through reasoning. We further analyze cases that deviate from this pattern and find them associated with behavioral failures such as poor evidence assimilation, motivating two targeted interventions: Evidence Assimilation Steering (EAS) and Evidence Review Steering (ERS). Building on these findings, we propose Probe-Gated Steering (PGS), which uses deviations in the task progress representation together with behavioral labels to train probes that detect likely failures online and selectively apply EAS or ERS. Extensive experiments validate the effectiveness of PGS in improving agent performance.

Primary area:
interpretability and explainable AI
Keywords:
LLM Agents, Long-Horizon Tool Use, Task Progress Representation, Activation Engineering

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_mEhoOpenReview ↗
Rating
3(+1)
Confidence
2
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper studies whether tool-use agents internally represent task progress. It identifies progress-sensitive directions using externally verified evidence and matched comparisons. It then proposes Probe-Gated Steering (PGS) to improve evidence assimilation and action selection. Experiments show improvements on two travel-planning benchmarks.

Critical strengths
  1. Meaningful research question and well-motivated analysis. The paper addresses an important question about how agents internally track progress during long-horizon execution. The analysis proceeds logically from identifying progress-sensitive representations to examining their evolution. Externally verified progress and matched comparisons provide a reasonable foundation for these findings.
  2. A reasonable probe-based method grounded in the findings. PGS naturally extends the analysis by detecting potentially problematic states and selectively applying targeted steering. Distinguishing evidence assimilation from evidence review gives the interventions clear motivations. The component ablations provide supporting evidence for this design.
Critical weaknesses
  1. The benchmark scores make the gains difficult to assess. Complete-task success is zero or very low, while Delivery Rate is already near saturation for several baselines. This combination makes the reported improvements appear modest in practical terms. Moreover, the best-of-two protocol, labeled pass@2, obscures single-run performance and may be sensitive to sampling variability. Pass@1 results, repeated evaluations, and confidence intervals are needed to establish whether the gains reliably exceed run-to-run fluctuations.

  2. Evaluation is limited to travel planning. The method targets general mechanisms of progress tracking and evidence integration, so its evaluation should extend beyond travel planning. Additional benchmarks, such as WebArena for web interaction or SWE-bench for coding, would test its broader applicability. Any other suitable long-horizon agent benchmark outside travel planning would also help address this limitation.

Questions for authors

See the weankness.

6 comments
AuthorsOpenReview ↗

Response to Reviewer mEho (1/2)

We appreciate your recognition of our work and your careful review and thoughtful suggestions. Below, we address the concerns with additional analyses and a cross-domain evaluation.

Q1. Single-run Performance and the Role of Pass@2

We originally adopted Pass@2 as a complementary evaluation protocol to reduce the variability of evaluation outcomes in long-horizon planning. These tasks involve many steps and are sensitive to local errors; on difficult tasks, Pass@1 scores can be very low and vary substantially across sampled rollouts, making comparisons based on a single rollout less stable. Best-of-two evaluation can partially mitigate single-rollout sampling noise and provide a more stable comparison between methods. Nevertheless, we agree that Pass@1 is important for understanding single-run performance and therefore report additional results below.

Additional Pass@1 results on DeepPlanning-Travel(all values in %):

ModelMethodDRCSPSCompositeCaseAcc
Qwen3-14BBase91.732.87.520.20.0
PGS94.236.09.222.60.0
Ministral-3-14BBase65.821.05.013.00.0
PGS71.730.18.319.20.0

PGS consistently improves the scorable trajectory ratio and all three plan-quality metrics under Pass@1. In particular, the Composite Score increases by 2.4 points for Qwen3-14B and 6.2 points for Ministral-3-14B. These results show that the improvements are also present under single-rollout evaluation, rather than arising solely from best-of-two selection. We will include more results in the revision and clarify the complementary roles of Pass@1 and Pass@2.

Q2. Interpreting Delivery Rate and End-to-End Planning Quality

We would like to clarify that the practical improvements of PGS are reflected in multiple complementary metrics, rather than Delivery Rate alone.

First, PGS improves Delivery Rate across all evaluated models. The gains are particularly notable for Ministral and Apriel, whose baseline delivery rates are relatively low (82.5% and 71.7%), with improvements of 4.2 and 5.8 percentage points, respectively. Importantly, PGS still yields gains for Qwen models with already high baseline delivery rates (97.5% and 99.2%), improving them by 1.7 and 0.8 percentage points, respectively.

Second, PGS improves overall itinerary quality beyond successful plan delivery. CS measures the commonsense plausibility and execution logic of itineraries (e.g., temporal arrangements, route continuity, and budget consistency), while PS measures satisfaction of explicit personalized hard constraints. Under Pass@1, PGS improves CS/PS by 3.2/1.7 points for Qwen3-14B and 9.1/3.3 points for Ministral-3-14B, yielding Composite Score gains of 2.4 and 6.2 points, respectively. These improvements demonstrate that PGS enhances not only whether a plan is delivered, but also the quality and constraint satisfaction of the resulting itinerary.

Furthermore, end-to-end success is not uniformly zero across our evaluation. On TravelPlanner, PGS improves Final Pass Rate under both protocols. For example, under Native, Qwen3-32B improves from 3% to 5%, and Ministral-3-14B from 0% to 2%; under ReAct, Ministral-3-14B improves from 2% to 4%.

We acknowledge that CaseAcc remains zero on DeepPlanning-Travel in our experiments. This benchmark imposes tightly coupled temporal, spatial, and budget constraints, where a single violation can invalidate the entire plan; its all-or-nothing CaseAcc is therefore substantially stricter than partial plan-quality metrics. This difficulty is also reflected in the benchmark's evaluation of frontier models. Our claim is not that PGS resolves all global planning constraints, but that it improves evidence assimilation and action selection, leading to measurable gains in plan quality and end-to-end success on TravelPlanner.

AuthorsOpenReview ↗

Response to Reviewer mEho (2/2)

Q3. Generalizability of the Method

Our existing results already demonstrate the framework's robustness across multiple settings: progress representations are validated across two models and two travel benchmarks, while PGS improves performance across models and both Native and ReAct protocols. We also observe gains on Chinese tasks (CP: 23.3 → 27.2). Ablations support the contributions of EAS and ERS, and show that targeted triggering outperforms random triggering (CP: 27.2 vs. 24.0). Moreover, the two travel benchmarks cover different constraint structures and difficulty levels.

We agree that evaluating additional planning domains is valuable for further assessing the framework's applicability. Within the limited rebuttal period, we conducted additional rollouts on DeepPlanning-Shop and completed both representation analysis and downstream PGS evaluation.

Shopping Planning involves product-attribute matching, multi-product selection, coupon constraints, and budget optimization, providing a distinct planning domain beyond travel-specific entities and constraints. The additional results are as follows.

Progress representation (Qwen3-14B, 263 held-out test pairs per anchor):

Anchor(v^E)(v^D)(v^P)
Entry90.1%76.0%89.7%
Decision86.3%86.7%87.1%

All directions achieve PairAcc substantially above chance (50%) at both anchors, including the shared progress direction.

Downstream PGS performance:

MetricPass@1 (Base → PGS)Pass@2 (Base → PGS)
Match Acc21.4% → 23.8%36.4% → 44.7%
Case Acc4.2% → 5.8%8.3% → 10.8%

Match Acc measures micro-averaged partial matching of required products and coupons, whereas Case Acc requires all ground-truth items to be matched. PGS improves both metrics under Pass@1 and Pass@2 evaluation, providing further evidence that the framework extends beyond travel planning.

More generally, the framework is not tied to travel-specific entities or constraints. It can be adapted to other tool-use domains by grounding progress in their verifiable task states and adapting the corresponding progress verifier and learned components. For coding and web/GUI agents, this would involve progress references grounded in code changes or browser/environment states, with appropriate handling of state revisions. We will clarify this scope and the required adaptations in the revision, and further explore these settings in future work.

Dear Reviewer mEho,

We sincerely appreciate your thoughtful assessment and, in particular, your recognition of the significance of our research question and the motivation behind our approach. We have carefully addressed the concerns raised in your review through additional Pass@1 results, further clarification of the evaluation metrics, and a new cross-domain evaluation on DeepPlanning-Shop.

We would like to draw your attention to our detailed rebuttal and respectfully ask that you carefully consider these additional results in reassessing the paper. As the discussion period is nearing its end, we look forward to hearing from you before it closes.

Best, Authors

Reviewer_cRNzOpenReview ↗
Rating
3(+1)
Confidence
3
Informativeness
2
Presentation
2
Soundness
1
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Paper summary

This paper analyzes whether LLM model's internal activation states reflect task progress during long-horizon tool use. The authors measure progress scores using a prescribed checklist of task requirements and identify internal activation signals that best correlates to the external scores. Building on this analysis, the proposed method learns to detect internal states associated with misinterpreting results from tool use or selecting unhelpful actions.. When such states are detected, it applies activation steering to guide the model toward better reasoning and action selection. Experiments on two travel-planning benchmarks show improved plan quality and valid plan delivery, though fully correct plans remain rare.

Critical strengths

The paper connects internal representation analysis with interventions that improve agent behavior. Matching states from the same task and turn, together with action-matching and shuffled-label controls, helps reduce some alternative explanations for the progress signal. Separating evidence assimilation from action selection also provides a useful way to study failures at different execution stages. Experiments across several models and ablations of the two interventions provide evidence that selective steering can improve planning performance.

Critical weaknesses

The progress reference is insufficiently specified and validated. The checklist is built from benchmark constraints and canonical target fields, but the complete construction and verification rules are not described in detail. Checklist sizes, the degree of automation, and the treatment of alternative valid solutions are also unclear. Since this reference supports direction extraction, deviation analysis, and probe-training example selection, these gaps affect several stages of the study.

Important details needed for reproducibility remain unclear. The paper does not fully explain the data and criteria used to select layers, the number of training samples, or the complete settings for each model. The paper also provides no code repository or release statement. Releasing the implementation, data splits, checklists, probes, and steering configurations would make the results easier to verify.

The evaluation covers only one problem domain. Both benchmarks involve gathering information and satisfying travel constraints. Tests on coding, web interaction, or embodied tasks are needed to assess whether the method works when progress can be revised or reversed. It is also unclear which components would require domain-specific reconstruction or retraining.

The paper follows a clear overall structure, moving from progress measurement to representation analysis and targeted intervention. However, repeated abstract terms make the method harder to follow than necessary. The distinctions between evidence coverage, internal progress signals, and actual task completion should be clearer. The paper should also better explain and support the link between the identified progress deviations and the gains from steering.

Questions for authors
  1. How exactly are the progress checklists constructed and verified for each benchmark? Please provide the decomposition rules, checklist-size distributions, automation procedure, and handling of alternative valid solutions. What evidence supports interpreting this measure as task progress rather than evidence coverage?

  2. Were the intervention layers selected using one benchmark, separately for each benchmark, or a pooled dataset? If selected on one benchmark, were they reused unchanged on the other? Please specify how PairAcc and EFA determine the choice and whether the implementation and complete configurations will be released.

8 comments
AuthorsOpenReview ↗

Response to Reviewer cRNz (1/3)

We thank you for the feedback and for recognizing the value of our work. Several concerns appear to rest on details already specified in the submission or on a different reading of our objective. We clarify these below and add the requested analyses and new experiments on an additional benchmark.

Q1. External Progress Checklist Construction and Verification

We would like to respectfully note that the checklist construction and verification rules are specified. Sec. 3.2 and Appendix A.2 (Eq. 11) already explicitly describe the procedure, including atomic decomposition, tool-observation matching, fail-closed verification of composite constraints, and monotonic progress updates, accompanied by a concrete benchmark-metadata example. We further clarify the implementation and provide additional statistics below.

  1. Construction and automated verification.

Our checklists are constructed programmatically from structured task constraints, metadata, and canonical target fields already provided by the benchmarks. Predefined benchmark-specific rules decompose these into equally weighted evidence items. At each turn, successful tool observations are matched against the required tool types, query arguments, and expected entities or conditions. Missing, failed, or ambiguous evidence leaves an item unresolved; composite constraints are verified fail-closed, and verified evidence accumulates monotonically.

The entire progress evaluation is deterministic and requires no additional LLM judge or API calls, manual per-task progress annotation, or changes to the agent's execution.

  1. Checklist-size statistics.

As illustrative examples, we additionally analyzed the checklists corresponding to a subset of the data used in our experiments.

BenchmarkTasksTotal itemsMeanMedianMin–MaxQ1–Q3
DeepPlanning-Travel1206015.0154–94–6
TravelPlanner1802,26012.56126–219–16

The automated verifier covers all 601 checklist items. Their per-task size distribution is: 4 items (51 tasks), 5 (33), 6 (26), 7 (5), 8 (4), and 9 (1). TravelPlanner statistics cover the 180 validation-task checklists.

Item-category distributions (count and proportion):

DeepPlanning-Travel (601 items)Count (%)TravelPlanner (2,260 items)Count (%)
Transport145 (24.1%)Transport leg540 (23.9%)
Hotel120 (20.0%)Accommodation by city360 (15.9%)
Attraction157 (26.1%)Attraction by city360 (15.9%)
Restaurant162 (27.0%)Restaurant by city360 (15.9%)
Budget17 (2.8%)Budget180 (8.0%)
——Cuisine148 (6.5%)
——Candidate cities120 (5.3%)
——House rule77 (3.4%)
——Room type64 (2.8%)
——Transportation51 (2.3%)
  1. Two concrete checklist examples.

To illustrate the actual decomposition and verification rules, we provide two checklists generated from benchmark metadata.

Example A: DeepPlanning-Travel, Task 2 (5 items)

ItemTarget evidenceAllowed tool(s)
TransportReturn train G729, matching date, route, and train numberquery_train_info
HotelJI Hotel Dalian Renmin Roadquery_hotel_info
AttractionQingniwaqiao Commercial Districtrecommend_attractions, query_attraction_details
AttractionDonggang Business Districtrecommend_attractions, query_attraction_details
RestaurantHaishilou Food Gardenrecommend_restaurants, recommend_around_restaurants, query_restaurant_details

Each item specifies its permitted tools and expected matching fields. The two attractions are verified independently rather than treated as a single requirement.

AuthorsOpenReview ↗

Response to Reviewer cRNz (2/3)

Example B: TravelPlanner, Validation Task 83 (12 items)

RequirementItemsVerification target
Candidate cities1Two candidate cities
Restaurants2Restaurant evidence for each city
Attractions2Attraction evidence for each city
Accommodation2Accommodation evidence for each city
Transport legs3Three required intercity transport legs
Room type1Private room
Budget1Feasible candidate within the 3,400 budget threshold
Total12

These examples illustrate how benchmark-specific requirements are instantiated as verifiable evidence items. They describe the checklist structure, not items already resolved by the agent. Resolution is determined separately from successful tool observations during execution.

  1. Scope and alternative valid solutions.

We emphasize that our progress reference is not intended to judge the validity of arbitrary alternative final solutions. Rather, it measures the accumulation of task-relevant evidence verified against explicitly defined benchmark constraints, providing a deterministic and consistent reference without subjective LLM judgments.

The verification rules are necessarily benchmark-specific, and valid alternatives outside the specified canonical matching rules may not be counted. Our analysis uses this reference for ordinal comparisons of verified progress, not as a measure of final-plan correctness. We will make this distinction more prominent in the revision.

Q2. Clarifying the Research Objective and the Role of External Progress

We believe this concern may not fully account for the central objective of our study: to investigate whether agents internally represent how far they have objectively progressed toward task requirements, rather than to assess their performance at every intermediate step. This requires an external progress reference independent of the agent's own judgments.

In our evidence gathering setting, acquiring and verifying task-relevant information is an essential and objectively verifiable dimension of task progress. Our deterministic checklist captures this accumulation and provides an ordinal reference for comparing progress across natural execution states and interactions, without requiring additional self-assessment. Step-level evaluations, by contrast, are often impractical, since explicit reports or plans may distort execution.

Importantly, this reference need not be equivalent to exact end-to-end task completion to serve our research purpose. Sec. 3.2 explicitly defines it as externally verified evidence progress, while Appendix A.2 further distinguishes it from final-plan quality. The distinction between external progress, internal representations, and final task completion is thus already part of our experimental design. In summary, we believe this clarification should address the concern raised here.

Q3. Reproducibility and Fixed Layer Selection

Many of the requested specifications are already provided rather than omitted. Secs. 4, 6–8 and Appendices B.1 and D.1–D.3 detail the matched-pair construction, data splits and sampling procedures, model configurations, prompts, probe training, and steering settings. For example, Appendix B.1 specifies the task split and held-out evaluation pairs, while Appendix D.3 reports the selected layers, probe regularization and thresholds, and intervention strengths and windows.

Regarding layer selection, we selected a representative layer once for each model during preliminary DeepPlanning-Travel/Native analysis, informed by training-set PairAcc and EFA, and kept that model-specific layer fixed across subsequent benchmarks and protocols without further layer search. Fig. 1 further shows that progress-sensitive signals remain stable across a broad range of middle-to-late layers rather than depending on a narrow optimum.

Similarly, Appendix D.3 explains that steering strengths, intervention windows, and probe thresholds are reused across settings without extensive model- or benchmark-specific tuning. This design reduces computational cost and, importantly, avoids relying on heavily optimized configurations for each evaluation setting, strengthening the comparability and credibility of our findings. We will consolidate these details and provide the exact training-sample counts in the revision. A more exhaustive analysis of layer and hyperparameter choices would be a valuable direction for future work.

AuthorsOpenReview ↗

Response to Reviewer cRNz (3/3)

Q4. What Links the Progress Deviations to the Gains From Steering?

In fact, this link is a central part of our paper, explicitly developed and supported across Secs. 4–8: (1) Representation identification (Sec. 4): Matched comparisons reveal internal directions sensitive to externally verified task progress. (2) Progress flow (Sec. 5): We trace how these representations evolve, finding that internal updates align with verified progress gains (EFA = 0.84). (3) Deviation and behavior (Sec. 6, App. Table 5): Deviations from this flow are associated with poorer evidence assimilation and unproductive actions. (4) Targeted interventions (Sec. 6, Fig. 3): EAS and ERS are designed and experimentally validated to mitigate these respective difficulties. (5) Online PGS (Secs. 7–8): Deviation consistency, combined with behavioral labels, directly determines probe training samples and weights (Eq. 10), enabling selective online interventions.

This connection is supported by explicit experimental evidence rather than merely conceptual motivation. Deviation cases exhibit higher rates of poor reasoning (46% vs. 20%) and unproductive actions (26% vs. 14%); targeted EAS/ERS interventions demonstrate behavioral recovery (Fig. 3); and the PGS experiments (Table 2) and ablations (Table 3) confirm the contributions of both interventions and selective triggering. Together, these results establish a coherent, empirically supported progression from internal representation analysis to behavioral intervention, a logical connection also acknowledged by other reviewers. We will make this connection more prominent in the revision.

Q5. Generalizability of the Method

Our existing results demonstrate robustness across two models and two travel benchmarks at the representation level, and across four models and Native/ReAct settings for PGS. We also observe gains on Chinese tasks (CP: 23.3 → 27.2). Ablations support the contributions of EAS and ERS, as well as the benefit of targeted over random triggering (CP: 27.2 vs. 24.0). The two travel benchmarks also cover different constraint structures and difficulty levels.

Within the limited rebuttal period, we conducted additional rollouts on DeepPlanning-Shop to further assess the framework's applicability beyond travel planning. This benchmark represents a distinct shopping-planning domain involving product-attribute matching, multi-product selection, coupon constraints, and budget optimization. The results provide direct evidence in this new domain:

Progress representation (Qwen3-14B, 263 test pairs per anchor):

Anchor(v^E)(v^D)(v^P)
Entry90.1%76.0%89.7%
Decision86.3%86.7%87.1%

All directions remain substantially above chance (50%) at both anchors, including the shared direction (v^P), indicating that progress-sensitive representations also emerge in shopping tasks.

Downstream PGS performance:

MetricPass@1 (Base → PGS)Pass@2 (Base → PGS)
Match Acc21.4% → 23.8%36.4% → 44.7%
Case Acc4.2% → 5.8%8.3% → 10.8%

Improvements are observed under both single-rollout (Pass@1) and best-of-two (Pass@2) evaluation. Match Acc measures micro-averaged partial matching of required products and coupons, whereas Case Acc requires all ground-truth items to be matched. These results further demonstrate that the analysis and intervention framework extends beyond travel-specific entities and constraints to a distinct tool-based planning domain.

The same analysis-and-intervention framework can be applied to other tool-use domains by grounding progress in their verifiable task states. The corresponding progress verifier and learned directions/probes can be adapted to each domain. For coding and web tasks, progress references should also account for reversible state transitions rather than assume monotonically accumulating evidence. We will clarify these adaptation requirements in the revision and further investigate these domains through future experiments.

Reviewer_rWT9OpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper investigates whether long-horizon tool-use agents internally represent task progress. Using an externally verified evidence checklist, it constructs progress-sensitive directions at the entry and decision boundaries and analyzes their evolution during execution. Motivated by observed deviations, the authors propose probe-gated activation steering and evaluate it on two travel-planning benchmarks.

Critical strengths
  • The paper addresses a meaningful question about agents’ internal states beyond final task performance, with an explicit, externally grounded definition of progress.
  • The analysis includes held-out tasks, matching by task and turn, same-action and shuffled-label controls, and task-cluster bootstrap uncertainty estimates for the main EFA result.
  • PGS yields consistent improvements across several models and execution settings. The component ablations provide useful evidence for the contributions of EAS and ERS.
Critical weaknesses
  • Matching by task and turn does not fully isolate progress from correlated variables such as context length. Section 4.1 and Appendix B.1 lack additional controls establishing whether PairAcc remains robust to these factors, or whether scores vary with turn index at equal progress.
  • The analysis does not explicitly separate progress from completed-item identity or completion order. Under the checklist definition in Section 3.2, different completed subsets can have equal progress, but the behavior of the proposed readout in these cases remains unclear.
  • Tables 2–3 provide evidence across protocols and languages, but the sensitivity of PairAcc and EFA to task prompts and interaction protocols is not directly examined. The robustness of the representation findings therefore remains less clear than that of the downstream performance gains.
  • The error analysis could be more informative. Appendix B.2 tests two progress-gap thresholds, but does not characterize ordering errors across progress-gap ranges or examine whether different models exhibit similar error patterns.
Questions for authors
  1. Section 4.1 and Appendix B.1 match states by task and turn. Could the authors additionally control for other variables correlated with progress, such as context length, and compare PairAcc before and after these controls? For states from the same task with equal progress but different turn indices, do their projections onto vPv_P remain correlated with turn index?

  2. Section 3.2 assigns equal progress to states with the same number of completed checklist items within a task. How does vPv_P in Eq. (4) behave when trajectories complete different subsets or follow different valid orders? For example, how do the projected scores compare for abcd versus efgh, and does PairAcc remain high for abc versus defg?

  3. The Native/ReAct comparison in Table 2 and the Chinese/English experiments in Table 3 provide some evidence of robustness. Could the authors further analyze how changes to task prompts and interaction protocols affect PairAcc, EFA, and the performance gains from PGS, using the same model and tasks? This would clarify the results’ dependence on the prompt and execution harness.

  4. Appendix B.2 compares PairAcc under progress-gap thresholds of 0.10 and 0.15. For the cross-model results in Table 1, could the authors further stratify ordering errors by the actual progress gap to determine whether errors concentrate on trajectory pairs with similar completion levels? Are these error patterns consistent across models?

5 comments
AuthorsOpenReview ↗

Response to Reviewer rWT9 (1/2)

We sincerely thank you for the positive recognition of our work and for the thoughtful, highly professional suggestions reflecting your deep consideration. These comments have helped us clarify the key analyses and strengthen the presentation, and we address each point in detail below.

Q1. Context length and turn index as potential confounds

  1. Context-length differences in the original pairs Our original pairs match task identity and turn index across rollouts. To further characterize context-length variation, we measured the absolute differences in Entry-prompt token counts across the available DeepPlanning-Travel pairs.
ModelMedian gap80th percentile90th percentileLonger-context acc.
Qwen3-14B9351,7892,32765.6%
Ministral-3-14B1,5583,5715,80858.0%

Most pairs exhibit relatively limited context-length differences. The longer-context accuracy measures how often the state with more context has higher checklist-based progress; it is above chance, but the advantage is modest. Thus, length alone is insufficient to account for the observed progress-sensitive readout.

  1. Fixed-direction evaluation with tighter length matching

For Qwen3-14B, we kept the original layer-25 directions vEv^E and vDv^D fixed and evaluated held-out pairs with increasingly tighter Entry-context length constraints:

Maximum context-length differenceEntry PairAccDecision PairAcc
512 tokens63.4%65.4%
1,024 tokens68.5%69.3%
2,048 tokens69.8%71.4%

PairAcc remains above chance under all three restrictions. Although tighter matching lowers the values somewhat, the fixed directions still retain ordering ability among more closely length-matched states, supporting that the readout is not reducible to context length alone.

  1. Complementary analysis with length-matched pairs

We also applied a 1,024-token Entry-context matching threshold during direction estimation, retaining the same task, turn, and progress-gap criteria (Δp≥0.10\Delta p\geq0.10). We evaluated the original and refitted directions on the same held-out 300 length-matched pairs:

DirectionEntry PairAccDecision PairAcc
Original67.7%69.7%
Refitted on length-matched pairs72.3%71.3%

Refitting yielded modest improvements at both anchors, providing a complementary assessment of progress readout under tighter context-length matching.

As an additional check, we fitted separate directions on a sign-balanced diagnostic set. Both training and test sets contained 150 pairs where the higher-progress state had a longer context and 150 where it had a shorter context.

Context length of the higher-progress stateTest pairsEntry PairAccDecision PairAcc
Longer15071.3%68.0%
Shorter15069.3%66.7%

PairAcc remains above chance in both conditions, including when the higher-progress state has a shorter context. This further suggests that the readout is not simply detecting longer prompts.

  1. Projection scores at equal progress across turns

To examine turn-related effects, we grouped states by task and progress, averaged projection scores at each turn, and computed within-group Spearman correlations with turn index. Only groups spanning at least three turn indices were included.

Grouping conditionGroups / tasksEntry ρ\rhoDecision ρ\rho
Same task and progress104 / 33−0.25−0.21
Same task, progress, and completed-item set112 / 33−0.28−0.23

The correlations are negative in both settings, including when the completed-item set is fixed. This provides no evidence of a positive turn-index trend at equal progress, although it does not establish complete invariance to execution history.

AuthorsOpenReview ↗

Response to Reviewer rWT9 (2/2)

Q2. Different completed-item subsets and completion orders

We evaluated the frozen layer-25 direction on the Qwen3-14B pair pool, grouping them by the Jaccard overlap of their completed-item sets, J(SA,SB)=∣SA∩SB∣/∣SA∪SB∣J(S_A,S_B)=|S_A\cap S_B|/|S_A\cup S_B|. Pairs were split at the median overlap (J=0.5J=0.5.

Item-set overlapPairs / tasksMedian Δp\Delta pEntry PairAcc [95% CI]Decision PairAcc [95% CI]
Low (J<0.5J<0.5)236 / 220.33379.7% [71.2%, 86.7%]83.5% [78.6%, 88.4%]
High (J≥0.5J\geq0.5)791 / 340.25070.5% [64.1%, 77.4%]70.7% [66.5%, 75.0%]

The low-overlap group includes 137 pairs with disjoint item sets (J=0J=0). CIs are based on 2,000 task-cluster bootstrap resamples. PairAcc remains well above chance even for low-overlap pairs, indicating that the direction retains progress-ordering ability across different item compositions. However, this group also has a larger median Δp\Delta p, so the difference between groups cannot be attributed to item overlap alone.

Importantly, equal progress does not imply identical evidence or hidden states: a,b,c,d\\{a,b,c,d\\} and e,f,g,h\\{e,f,g,h\\} both yield p=0.5p=0.5 and therefore do not form an ordered PairAcc pair. In contrast, a,b,c\\{a,b,c\\} and d,e,f,g\\{d,e,f,g\\} yield p=3/8p=3/8 and 4/84/8, respectively, forming an ordered pair. Thus, our analysis tests progress ordering across different item compositions, not invariance to item identity or completion order.

Q3. Sensitivity to the interaction protocol

  1. PairAcc under ReAct

We evaluated Qwen3-14B on DeepPlanning-Travel under ReAct, fitting a layer-25 shared direction with the same Entry/Decision anchors and pair-normalized contrastive procedure. On a 300-pair held-out sample spanning 35 tasks, it achieves 77.0% Entry and 73.7% Decision PairAcc.

ProtocolPairsEntry pooled / task-macro PairAcc [95% CI]Decision pooled / task-macro PairAcc [95% CI]
Native100076.6% / 73.8% [67.7%, 78.1%]75.1% / 74.5% [70.1%, 77.5%]
ReAct30077.0% / 77.4% [69.8%, 84.3%]73.7% / 73.4% [65.3%, 81.0%]

The task-bootstrap differences between ReAct and Native are small for both Entry and Decision, and both difference intervals include zero. Thus, progress ordering remains above chance under both protocols, with no clear difference between them.

  1. Protocol differences and PGS performance

Native allows one tool action per assistant turn, whereas ReAct interleaves Thought, Action, and Observation. In the existing Table 2 Pass@2 CP results, PGS improves both models under both protocols: Qwen3-14B from 22.8 to 27.2 (+4.4 points) under Native and 26.3 to 29.1 (+2.8) under ReAct; Ministral-3-14B from 18.1 to 23.9 (+5.8) and 21.9 to 27.0 (+5.1), respectively. Together with the ReAct PairAcc results above, these findings provide complementary evidence of robustness at the representation and downstream-performance levels.

Q4. Ordering errors across progress-gap ranges

To examine PairAcc errors across progress gaps, we separately sampled held-out pairs from the larger pool and stratified them by progress gap, using the frozen Entry and Decision directions (Qwen3-14B: layer 25; Ministral-3-14B: layer 30) without refitting.

ModelProgress gapPairsEntry PairAcc [95% CI]; errorDecision PairAcc [95% CI]; error
Qwen3-14BMedium [0.15,0.25)38574.0% [65.2%, 83.4%]; 26.0%68.1% [62.6%, 74.3%]; 31.9%
Qwen3-14BLarge (≥ 0.25)50170.1% [61.9%, 77.6%]; 29.9%77.2% [71.8%, 82.5%]; 22.8%
Ministral-3-14BMedium [0.15,0.25)4881.3% [69.7%, 93.8%]; 18.8%77.1% [61.5%, 93.8%]; 22.9%
Ministral-3-14BLarge (≥ 0.25)8466.7% [55.8%, 78.8%]; 33.3%79.8% [70.0%, 87.8%]; 20.2%

The small-gap bin [0.10,0.15) is omitted due to limited samples. Error patterns vary across models and anchors: Entry errors increase with larger gaps for both models, while Decision errors decrease for Qwen3-14B but remain nearly stable for Ministral. Thus, these results do not directly establish a consistent cross-model pattern, and the sparse small-gap results do not support reliable conclusions for that range.

Dear Reviewer rWT9,

We appreciate your careful review and the opportunity to clarify the points raised. We have conducted additional analyses addressing your suggestions, including further controls for context length, turn index, and item-set overlap, as well as evaluations under the ReAct protocol.

As the discussion period is nearing its conclusion, we would appreciate knowing whether our responses have addressed your concerns. We look forward to hearing from you.

Best, Authors

Comments on the paper

1 comment

Dear Chairs and Reviewers,

We sincerely appreciate the time and effort you have devoted to our paper. We thank the reviewers for recognizing our contributions and conducted additional analyses and experiments during the rebuttal to address their concerns. Below, we summarize the key strengths of our work and our responses.

(A) Key Strengths Recognized by the Reviewers

(1) An important research question and a new perspective on agent execution. Reviewers rWT9 and mEho recognized the significance of investigating how LLM agents internally track task progress beyond final outcomes. We examine whether internal representations reflect externally verified progress during long-horizon tool use.

(2) Carefully controlled representation-level analysis. Reviewer rWT9 highlighted our held-out evaluation, task-and-turn matching, and controls for task identity and execution stage. We identify progress-sensitive directions at both Entry and Decision and trace their evolution through a shared progress representation.

(3) A coherent connection between representation analysis and behavioral intervention. Reviewers cRNz and mEho recognized the connection from internal progress representations to behavioral diagnosis and targeted intervention. EAS and ERS address distinct execution failures, motivating the online Probe-Gated Steering (PGS) framework.

(4) A practical intervention framework with consistent improvements. Reviewers rWT9 and cRNz acknowledged the effectiveness of PGS and its ablations, while mEho recognized its probe-based design. PGS improves planning quality and execution robustness across models, benchmarks, and protocols.

(B) Responses to the Reviewers' Main Concerns

(1) Representation robustness and potential confounding factors (Reviewer rWT9). We tested whether the representation findings could be explained by context length, turn index, completed-item identity, or interaction protocol. Length-matched and sign-balanced evaluations remain above chance; even disjoint completed-item pairs achieve 79.7%/83.5% PairAcc at Entry/Decision. Under ReAct, PairAcc remains comparable to Native (77.0%/73.7%). We also stratified ordering errors by progress gap across Qwen3-14B and Ministral-3-14B, strengthening the robustness of our findings. Reviewer rWT9 highlights these controls and recognized our response.

(2) External progress construction and reproducibility (Reviewer cRNz). Checklist construction and verification are already specified in Secs. 3.2/A.2, including atomic decomposition, tool-observation matching, and composite-constraint checks; we cite these details and add statistics/examples. The paper defines the checklist as measuring externally verified task-relevant evidence progress and fixes model-specific layers across evaluations. This concern therefore addresses established methodology rather than a substantive gap.

(3) Connecting progress deviations to intervention gains (Reviewer cRNz). The empirical and logical chain underlying PGS is already established: progress-sensitive directions track verified progress (EFA = 0.84); deviations correlate with poorer reasoning and unproductive actions; and EAS/ERS target these failures. The existing evidence already supports the PGS design, making this concern primarily an issue of interpretation.

(4) Single-run performance and practical evaluation (Reviewer mEho). We directly addressed mEho's concern that Pass@2 might obscure single-run performance. We clarified Pass@2 as a complementary best-of-two protocol to mitigate sampling variability, and added Pass@1 results: PGS improves Composite Score from 20.2→22.6 for Qwen3-14B and 13.0→19.2 for Ministral-3-14B, with consistent gains in DR, CS, and PS. We further clarified the practical significance of these metrics and reported Final Pass Rate improvements on TravelPlanner under both Native and ReAct protocols.

(5) Applicability beyond travel planning (Reviewers cRNz and mEho). Our existing results demonstrate robustness across two models, two travel benchmarks, and Native/ReAct protocols. To further test cross-domain applicability, we conducted additional representation and PGS experiments on DeepPlanning-Shop. The shared progress direction achieves 89.7%/87.1% PairAcc at Entry/Decision, while PGS improves Match Accuracy from 21.4% to 23.8% under Pass@1 and from 36.4% to 44.7% under Pass@2. These results provide additional evidence that the framework is not specific to travel planning, directly addressing the concerns raised by cRNz and mEho.

We sincerely thank all reviewers for their constructive feedback. We believe the additional analyses, clarifications, and cross-domain experiments substantially strengthen our contributions and address the key concerns raised during the discussion. We respectfully ask that the additional evidence be considered in the final assessment of our paper.

Best regards, The Authors

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