acceptodds
Under review as a conference paper at ICLR 2027

How Strongly Should Task State Influence an LLM Agent?

Abstract

Long-horizon assigned work requires an LLM agent to track the state of a task: which steps are done, blocked, cancelled, or open to repetition. Agent systems either keep this state as text in the prompt and rely on the model to read that text, or move the state into a module that enforces it, and each system is evaluated as a whole, so no one knows how much reliability comes from the state being shown, told, or enforced. We fix the task rules, the model, and paired episodes and vary how strongly task state reaches the agent: a raw transcript, an exact checklist, per-turn directives from a state machine compiled from the brief and advanced only by execution receipts, or an enforcement gate on that machine that refuses state-violating actions. Every episode is scored by exact payload matching against dynamic ground truth. Across three models, two reasoning regimes, and two domains, four findings hold without per-turn reasoning: displaying accurate state is unreliable, an unverified ledger the agent writes itself beats an accurate checklist it is shown, directives help in proportion to the model's obedience, and enforcement needs no obedience but is bounded by the correctness of its state and by the matcher that maps requests to steps. Per-turn reasoning at a 235B agent compresses these separations without repairing the text rungs. The same gate, compiled from -bench's airline policy, raises a 235B agent's pass from 0.39 to 0.54 and changes nothing for a 35B agent that rarely violates the policy. On PM-Bench, where acting turns on recognizing a cue rather than on state, showing the record is the best rung. It matches or beats both gates and reverses the ledger-over-checklist finding, and enforcing the matcher's judgement drops a 35B agent below its raw transcript. Enforcement pays when failures are state-decidable and frequent, and hurts when the gate's judgement is wrong.

Primary area:
foundation or frontier models, including LLMs
Keywords:
LLM agents, task state, long-horizon tasks, enforcement, tool use, agent evaluation

Reviews

Among:
Shape:
1234this paper, Top 15%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_N5AbOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper investigates how task state should influence an LLM agent during multi-step, long-horizon task execution. To answer this question, the authors introduce a four-tier "state-coupling ladder": (1) raw conversation transcripts, (2) accurate text checklists, (3) per-turn directives generated from a compiled task-state machine, and (4) runtime enforcement gates that block state-violating actions. Through extensive evaluations using synthetic task episodes with verifiable execution receipts, real-tool harnesses, and external benchmarks (such as τ2\tau^2-bench and PM-Bench), the paper demonstrates that stronger state coupling generally improves strict task success rates (e.g., rising from 0.380.38 for raw transcripts to 0.980.98 for enforcement gates in the baseline Qwen3-235B no-thinking setting). Furthermore, the authors provide a nuanced analysis showing that while enforcement is beneficial when violations are state-decidable, it can become detrimental when state compilation errors or request matcher misalignments occur.

Critical strengths
  1. Well-Defined and Measurable Problem: The paper formalizes task lifecycle errors and evaluates execution through verifiable receipts rather than relying solely on noisy LLM-as-a-judge metrics. The use of paired episodes, confidence intervals, and corrected statistical tests provides a solid empirical foundation.
  2. Valuable Diagnostic Analysis and Negative Results: Rather than stopping at "stronger enforcement is always better," the authors investigate failure channels, perform state-corruption experiments, test request wording perturbations, and highlight PM-Bench negative results where runtime enforcement hinders performance. This yields a nuanced, conditional understanding of when state-driven controls are effective.
  3. Comprehensive Empirical Scope: The study covers multiple task scales, model families, reasoning regimes (Thinking vs. No-think), and external benchmarks (τ2\tau^2-bench and PM-Bench), accompanied by transparent artifact disclosure plans.
Critical weaknesses
  1. Confounding Variables Along the State-Coupling Ladder: The four tiers do not isolate coupling strength as a single variable. The text checklist utilizes generator-provided oracle state, whereas the directive and enforcement gates rely on LLM-compiled states and an auxiliary request-matching module. Consequently, performance gains between tiers conflate state accuracy and semantic parsing capabilities with pure state-coupling strength. A rigorous isolation of state quality and request matching is missing.
  2. Incomplete Enforcement Guarantees (State-Bound vs. Request-Bound): The main synthetic experiments employ state-bound enforcement, which blocks actions only if they violate state machine rules (e.g., executing a completed or blocked step). However, it permits actions that are state-legal but unrequested by the user. Because unrequested execution is defined as an error by the authors, the reported high success rates (e.g., 0.980.98) do not equate to full behavioral correctness.
  3. Limited External Validity and Synthetic Task Bias: The main evaluation relies on synthetic procurement and release tasks characterized by fixed episode lengths (44 turns) and pre-scripted probes. While controlled, this narrow task distribution leaves open whether the findings generalize to natural, unconstrained user requests, multi-task parallel workflows, and messy real-world tool environments.
  4. Sensitivity to Reasoning Regimes and Scoring Rules: The interaction between reasoning budgets (Thinking vs. No-think) significantly compresses architectural gaps, indicating that model capability heavily mediates the necessity of strict state coupling. Furthermore, under alternative scoring rules (such as decline-aware scoring), the marginal benefits between directive and enforcement gates are notably less pronounced.
Questions for authors
  1. Disentangling State Quality and Request Matching: Can the authors provide controlled cross-comparisons where all tiers share a uniform state source (both oracle and LLM-compiled) and a uniform request-resolution mechanism? Does the reported ordinal ranking persist under these controls?
  2. Request-Bound Enforcement on Main Benchmark: Why was state-bound enforcement primarily used in the main benchmark when unrequested actions violate correctness? Can the authors report request-bound enforcement results on the main task episodes, including detailed error breakdowns?
  3. Robustness to Natural Language and Reasoning Modes: How robust are the findings when tasks are driven by independent, natural language user requests rather than template-derived phrasing? Do the benefits of enforcement hold across matched reasoning budgets within the same model family?
  4. External Benchmark Vetting Details: For the τ2\tau^2-bench evaluation, to what extent were the rules vetted or adjusted using gold trajectories before final testing? Please clarify how much of the performance gain stems from zero-shot policy compilation versus post-hoc reference tuning.
Reviewer_4bgiOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
2
Soundness
3
Read review
Paper summary

The paper examines how well LLM agents can manage multi-step tasks over long conversations, where users might change the plan, cancel tasks, or ask the agent to repeat something already completed. The paper investigates whether a separate system to manage task states can improve agent performance, and how strongly it needs to control the agent’s behaviour, for example, via a raw transcript, a checklist, a directive gate, and an enforcement gate. The results show that simply providing the task state as a checklist does not always help much. Agents can have access to the correct information and still make mistakes. Explicit directives lead to much better performance, while enforcement generally performs best. For example, in one setting, success increases from 38% with the raw transcript to 55% with the checklist, 84% with directives, and 98% with enforcement. However, the gap between directives and enforcement shrinks with stronger models and depends on instruction clarity and response evaluation.

Critical strengths
  1. One strength of the work is that it isolates the effect of different ways of managing task state. The same models and projects are used across the four approaches, which makes it possible to compare whether showing the state, giving instructions, or enforcing them actually improves performance.
  2. Another strength is the evaluation setup. The authors generate projects where the correct task state is known and use execution receipts, rather than another LLM, to evaluate whether the agent performed the correct action.
  3. The paper also extends beyond the main testbed by evaluating the approaches on two external benchmarks. This is useful because the findings are not entirely consistent across settings. In particular, the results show that enforcement helps when rules are clearly defined, but can hurt performance when deciding whether to execute a task requires interpreting more ambiguous language.
Critical weaknesses
  1. One limitation is that the main experiments use artificially generated projects with a predefined set of tasks and relatively clear instructions. Additionally, results on other benchmarks vary.
  2. A more important limitation is that enforcement depends on the system correctly understanding both the project and the user’s request. If the task-state machine incorrectly identifies a dependency, it might block an allowed action or allow a blocked one. Similarly, if the system incorrectly matches a user request to a task, it may give the agent the wrong instruction.
  3. There is also some uncertainty about how much additional benefit enforcement provides over directives. In one real-tool experiment, the enforcement gate did not actually block any tool calls, and its performance was almost identical to the directive approach. The paper also reports that some differences between directives and enforcement are no longer statistically significant under an alternative scoring method.

Overall, this suggests that managing task state outside the conversation can improve how reliably LLM agents handle multi-step projects. However, it is unclear whether the same improvements hold in less structured, real-world settings.

Questions for authors

None

Reviewer_ZzUsOpenReview ↗
Rating
3(+1)
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper studies how task state should guide the actions of LLM agents. It compares four settings: conversation history alone, an explicit task checklist, instructions derived from task state, and programmatic enforcement that blocks invalid actions. The experiments examine repeated execution, unmet dependencies, cancelled tasks, and user revisions, with additional evaluations using tools, τ²-bench, and PMbench. The results show that providing accurate state does not always lead to correct behavior. Explicit instructions often improve performance, while enforcement can further reduce invalid actions when the underlying state and rules are correct. However, incorrect state or misunderstood requests can cause valid actions to be blocked and reduce task completion. The paper is primarily an empirical study of when these approaches help and where they fail.

Critical strengths
  1. The paper addresses a clear and practical question. Even when an agent remembers the task state, it may not act accordingly. The paper compares four approaches: providing only the conversation history, showing a task checklist, giving explicit instructions about what to do, and using a program to block invalid actions. These comparisons help explain why telling an agent that a task is complete can produce different results from preventing it from executing that task again.

  2. The experiments are extensive and examine several factors that could affect the results. Beyond the main comparisons, the authors test task size, dependencies, prompts, memory methods, paraphrased requests, and incorrect state. They also include tool-use experiments and evaluations on external benchmarks. The authors further examine whether the scoring procedure mistakenly counts task identifiers in refusal messages as executions. These checks increase confidence in the results and help explain which factors affect them.

  3. The paper reports and analyzes cases where the approaches fail. The authors examine incorrect restrictions caused by faulty state, valid actions being blocked, and requests being misunderstood. Enforcement does not significantly improve performance in some experiments and can reduce performance on PMbench. These findings show that the benefits of enforcement depend on state accuracy, the suitability of the rules, and the system’s ability to interpret user requests correctly.

Critical weaknesses
  1. Direct comparisons with the closest existing methods are missing. The authors discuss FlowAgent, LedgerAgent, and Compile, Then Page, and explain that this paper focuses on constructing task state from user descriptions, handling user revisions, and distinguishing different execution errors. These are meaningful differences. However, the experiments mainly compare the authors’ own configurations. Although memory methods such as Mem0 are evaluated, closely related methods for state management and execution control are not directly tested. It therefore remains unclear whether the same problems occur in those systems and whether their mechanisms can mitigate them. Comparing one or two of the closest methods under the same model and task conditions would strengthen the paper.

  2. The main results rely on a limited set of models. Most systematic experiments use the Qwen family, while DeepSeek is evaluated in only some settings. The paper does test different models and reasoning configurations, but the coverage is uneven and does not establish how broadly the findings apply. In particular, the gap between explicit instructions and programmatic enforcement may depend on a model’s instruction-following ability. More complete comparisons across model families would help establish the scope of the conclusions.

  3. Evaluation on external tasks remains limited. The authors include tool-use experiments, τ²-bench, and PMbench, but most evidence still comes from generated tasks with scripted interactions. The main method comparisons on τ²-bench focus on the airline domain, while the PMbench evaluation uses a single week of tasks. Repeated runs on that week do not provide additional task diversity. These experiments are useful, but further evidence is needed to establish whether the findings hold across more domains, tool environments, and complex user interactions.

  4. State repair has not been evaluated through complete task runs. The authors analyze how incorrect state causes omissions or blocks valid actions. Appendix D.4 also examines whether execution records can restore the correct state. However, this analysis recomputes decisions from existing logs without allowing the agent to continue the task after repair. It shows that some incorrect instructions can be corrected, but does not establish whether repair restores task progress or prevents subsequent omissions and repeated executions. Complete runs with and without repair, reporting final task completion rates, would provide more direct support for the paper’s recommendations on handling incorrect state.

Questions for authors

please ref to the weakness

1 comment

Thank you for the additional experiments. The comparison with FlowAgent and the LedgerAgent-style baseline largely address my concern about prior work. The Llama and Mistral experiments also address my concern about model coverage. In both cases, explicit instructions worked about as well as enforcement, and I appreciate that you revised the paper’s claims accordingly. The complete runs with and without state repair resolve my fourth concern by showing that repair improves final task completion. The additional PM-Bench weeks and the telecom experiments broaden the evaluation, though evidence from real user interactions remains limited. These results answer most of my concerns and give me more confidence in the revised conclusions. I will raise my rating from weak reject to weak accept.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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