- Rating
- 3
- Confidence
- 4
- Informativeness
- 2
- Presentation
- 3
- Soundness
- 2
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Paper summary
This paper identifies generator-induced artifacts in replayed real samples as a potential source of bias in face forgery detectors. To address this issue, it proposes a dynamic generator update strategy, a domain-aware fast training scheme, and a new loss function for detector learning. Together, these components aim to mitigate domain confusion between replayed samples and real data arising from limitations of the replay generator.
----- after rebuttal ----- Response addresses most of my concerns. Thus, I keep the original rating of weak acceptance.
Critical strengths
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The motivation is clear and addresses a common practical challenge in generative replay for face forgery detection.
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The experiments are comprehensive, with ablation studies providing evidence for the contribution of each component.
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Under the assumptions considered in the paper, the proposed loss appears effective in reducing the influence of generator-induced artifacts on the detector.
Critical weaknesses
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The introduction’s claim of being the first to explore the feasibility of generative replay for face forgery detection would benefit from more precise positioning relative to prior work. Existing applications already provide evidence of its feasibility, whereas this paper’s contribution appears to lie primarily in identifying and addressing a specific limitation of this approach.
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The claim that replayed fake samples have no significant effect on detection performance, regardless of the replay generator, and that the main issue stems from replayed real samples is not sufficiently supported. RS Loss appears to suppress the influence of generator-induced artifacts in both replayed real and fake samples. Its effectiveness therefore does not, by itself, establish that replayed real samples are the primary source of the problem. Separate analyses of the two sample types would help substantiate this claim.
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The use of centroid distance as a measure of confusion risk requires further justification, particularly the assumed positive relationship between distribution separation and confusion risk. Although the proposed explanation concerns interactions between generator-induced artifacts and forgery traces, centroid distances may also reflect semantic content and other unrelated features. Additional analysis would help establish whether this measure reliably captures the intended source of confusion.
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The dynamic update strategy places greater emphasis on historical data when the measured discrepancy is large, while the generator must also adapt to new data. The effect of this potentially competing objective on training stability and convergence remains unclear. Further discussion and empirical evidence would help demonstrate how the strategy balances historical knowledge retention with adaptation to new distributions.
Questions for authors
see weakness
4 comments
Response to Reviewer 7mu1 (Part 2/2)
W3. Validity of centroid distance as a confusion proxy
Response. DC Score is computed in the detector’s own feature space, where the real and fake labels are actually applied, so the distance it reports is a separation measured where the decision is made. The smaller that separation, the less room a single boundary has to keep the two groups apart, and the more often the same features are pulled toward opposite labels; that is the confusion risk the score tracks. It is not a calibrated measure of overlap, since the features also carry identity and semantics and two centroids do not describe a distribution’s shape. The score is therefore used to order tasks, not to quantify overlap.
(1) Empirical evidence for the proxy
Two analyses provide complementary evidence:
- Replay replacement. The smaller-distance DDPM transition incurs a much larger generated-real replacement loss than the larger-distance WDF transition under both fake-replay conditions, using the same detector checkpoint and historical replay. Since the incoming task changes, this is evidence from two transitions rather than a general correlation or proof of the source of the distance.
- Distance alternatives. Table 5 reports average AUCs of 92.05 for DCS-Cos + RS-Cos and 92.91 for DCS-Cos + RS-L2, compared with 94.98 for DCS-L2 + RS-Cos. These end-to-end alternatives support the feasibility of angular measures, but do not by themselves isolate feature magnitude or establish that the score directly measures overlap.
Revision location: Section 3.2 (DC Score), Table 5 (distance ablation).
W4. Stability and the historical/current-data trade-off
Response. Adaptation is task-level: the score is computed at the task transition, and its resulting weight is held fixed during that task. Thus, the method does not introduce iteration-by-iteration changes in the coefficient, although the generator’s parameters and optimization losses still evolve normally. A larger score gives the fake-generator objective more weight on historical generated fakes; a smaller score gives more weight to current fakes. The real generator follows its separate, unweighted update objective. Across Protocol 1 the coefficient spans 0.2245 to 0.9980, so both regimes are exercised in the main experiments.
The adaptive-weight ablation compares adaptive weighting with fixed scores: average AUC is 95.74 with adaptation, versus 93.72 and 93.12 for fixed scores 0.5 and 0.1. The learning-behavior figure compares the training trajectories with and without domain-aware fast training. Together, these support the empirical value of the task-dependent trade-off.
Revision location: Section 3.3 (generator update), Table 2 (weight ablation), Figure 5 (generator learning), Table 4 (P1 scores).
Thank the authors for providing a detailed response that addresses most of my concerns. Thus, I keep the original rating of weak acceptance.
Thank You and Further Discussion
Dear Reviewer 7mu1,
Thank you for your encouraging feedback and continued support. We are pleased that our detailed responses have addressed most of your concerns, and we sincerely appreciate your careful consideration of our work.
Could you please share which specific concerns remain, or which aspects you feel would benefit from further clarification or supporting evidence? We would greatly appreciate the opportunity to discuss these points with you and address them more fully. We hope that this further exchange can help resolve any remaining reservations and strengthen your confidence in our work.
Thank you again for your time and constructive feedback.
Response to Reviewer 7mu1 (Part 1/2)
Thank you for the constructive suggestions on positioning, replay asymmetry, and adaptive control. We address the individual claims and their supporting evidence below.
W1. Positioning of the generative-replay claim
Response. We agree that the positioning should emphasize the limitation of replay, rather than imply that generative replay has not previously been shown to be feasible in related applications. A detector is required to distinguish real and fake content, while both replay domains are produced by a generator. Consequently, generated-real replay may introduce synthetic cues into real-side supervision, especially when those cues relate closely to the incoming forgery. Dual-CARE identifies this domain-confusion issue and uses the same task-level score to adapt generator training and detector supervision.
We have revised the opening discussion and the first contribution of the Introduction to describe the work as a systematic investigation of generative replay for incremental face forgery detection, with the identification and mitigation of domain confusion as its specific contribution. The priority claim is now stated only to the extent the literature comparison supports.
Revision location: Introduction (contribution positioning), Section 2 (motivation).
W2. Separate effects of generated-real and generated-fake replay
Response. We agree that the RS Loss ablation alone cannot attribute the effect to either replay class. We therefore use a four-way replay replacement comparison with all Dual-CARE components disabled. Each replacement is measured against the actual-real/actual-fake reference for the same incoming task. A uses actual historical real and fake samples; B replaces real replay only; C replaces fake replay only; and D replaces both. Δ denotes the change in average AUC relative to A, in percentage points.
Large-distance case: LDM → DFDCP → SDv21 → WDF; DC distance = 3.25.
Small-distance case: LDM → DFDCP → SDv21 → DDPM; DC distance = 0.26.
(1) Effects of replacing each replay class
The two controls show the same pattern:
The larger generated-real effect in the tested DDPM transition is visible under both fake-replay conditions and does not depend on RS Loss.
(2) Why the two replay classes differ
The label relationship offers a motivation for this asymmetry: a replay-generator artifact in generated real can be associated with the real label even when similar cues occur in current fakes. For generated fake, the fake label and synthetic cues are aligned, although reliance on generator-specific shortcuts remains possible.
Revision location: Section 2 (replay asymmetry), Section 4.8 (controlled replay replacement) and Table 6.