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- Informativeness
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- Presentation
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Paper summary
The paper constructs Pareto sets over model configurations using source-based likelihoods for public benchmark data. It recovers task success histograms from aggregate pass@k statistics, studies uncertainty and dependence in frontier membership, and illustrates switching decisions and value-of-information calculations under certain scenarios.
Critical strengths
- Recovering task success histograms from published aggregates makes otherwise unavailable heterogeneity analysis possible. The comparison with a Binomial model demonstrates why treating repeated trials as independent can inflate precision.
- The paper investigates the limitations of its inference through prior sensitivity, alternative dependence structures, and a paired trial-level panel. The temporal assessment is also useful, as it identifies which missing data prevent stronger conclusions instead of fitting unsupported dynamics.
Critical weaknesses
- Some frontier probabilities are sensitive to uncertainty omitted from the primary analysis. In Table 12, Grok 4.6's membership falls from 0.964 to 0.683 under only 2% log-scale perturbations of cost and duration. Also, the -bench likelihood omits within-cell sampling correlations despite available paired task rows (Appendix B), potentially attributing sampling dependence to workload variation. The conclusions should reflect more clearly these sources of uncertainty.
- The demonstrated contribution is overstated in relation to the lifecycle framing. No temporal model is fitted, and switching results depend on assumed cost and transport scenarios. Much of the framework uses Pareto and decision-theoretic methodology. Its value therefore comes from the archival analysis, with limited validation of improved lifecycle decisions.
Questions for authors
- Does the -bench tradeoff probability remain similar when the likelihood includes the estimated within-cell sampling covariance?
- After propagating cost and duration uncertainty, what are the probabilities that the configurations discussed are Pareto-optimal but are never optimal for any weighted averaged of the objectives?
8 comments
CYQc (2/5): probability of being Pareto-optimal but never optimal for a weighted average (Q2)
Q2: “After propagating cost and duration uncertainty, what are the probabilities that the configurations discussed are Pareto-optimal …”
The scalarisation result survives full propagation of cost and duration uncertainty. GPT-5.6 Terra is a frontier member in almost every draw yet is optimal for a weighted average in a minority of them.
On each posterior draw, a frontier member is supported if it maximises some nonnegative weighted sum of completion, negative cost and negative duration (checked by linear programming). Every supported configuration is a member, so the probability of being a member but never optimal for a weighted average is membership minus support. The Monte Carlo standard error is at most 0.005.
| configuration | target | membership | supported | member but unsupported |
|---|---|---|---|---|
| GPT-5.6 Terra | C66 | 1.000 | 0.093 | 0.907 |
| GPT-5.6 Terra | P66 | 0.984 | 0.211 | 0.773 |
| Opus 5 | C66 | 0.769 | 0.037 | 0.732 |
| Opus 5 | P66 | 0.792 | 0.378 | 0.415 |
| Grok 4.6 | C66 | 0.391 | 0.000 | 0.391 |
| Grok 4.6 | P66 | 0.153 | 0.002 | 0.151 |
C66 is the observed 66 tasks and P66 a new 66-task workload. Terra is likely a member under every estimator and is rarely optimal for a weighted average, so a weighted-average ranking would rarely put it first. For Opus 5 the answer depends on the target, and for Grok 4.6 the unsupported probability is mostly its membership, which reply 1/5 shows is undetermined. These model-based probabilities carry the narrow cost and duration intervals found in the known-truth test, most visibly near a dominance boundary. All configurations are in revised App. E.11.
CYQc (3/5): tau3-bench within-cell covariance (W1, Q1)
W1 (covariance clause): “Also, the τ³-bench likelihood omits within-cell sampling correlations despite available paired task rows (Appendix B), potentially attributing sampling dependence to workload variation. The conclusions should reflect more clearly these sources of uncertainty.” Q1: “Does the τ³-bench tradeoff probability remain similar when the likelihood includes the estimated within-cell sampling covariance?”
Yes, it changes by at most 0.002. Inferring the 3-by-3 within-cell covariance for completion, cost and duration (Wishart likelihood, LKJ correlation prior) gives a trade-off probability of 0.9757, against 0.9755 with the covariance plugged in as known and 0.9738 for the paper's likelihood pooled over 16 predictive replicates. The largest difference from the submitted likelihood is 0.002, and the quality heterogeneity scale moves from 3.40 to 3.16 percentage points. The comparison is model-based, and the Gaussian task law approximates per-task quality differences that take three values. The revised conclusions report the τ³-bench trade-off with the covariance inferred and state that this comparison is model-based (revised App. E.12).
CYQc (1/5): Table 12 and the fragility of Grok 4.6 (W1)
Table 12 is the paper's sensitivity analysis, and the trial data confirm what it showed. Grok 4.6 sits on a dominance boundary, its membership depends on the estimator and the target workload, and the trial-level estimates fall well below 0.964, so the revision reports it as undetermined.
The submitted model treats cost and duration as fixed, so a 2% perturbation of those coordinates moves Grok 4.6 from 0.964 to 0.683. Trial records now measure cost and duration per attempt on the same 66 tasks. The table gives membership probabilities from the model for the observed 66 tasks (C66) and for a new 66-task workload centred on the observed panel (P66), and bootstrap frequencies from resampling aligned tasks, either from the observed panel (plain) or for a new workload (predictive, added post hoc).
The frontier as a whole changes little: its expected size is 7.75 under the submitted model and 7.1 to 7.4 under every trial-level estimator. The task-paired trial model carries cost and duration uncertainty in every draw, so the 2% perturbation that moved the submitted model barely moves Grok 4.6 (P66 0.153 to 0.154, C66 0.391 to 0.394).
The remaining discrepancy comes from cost and duration. On datasets resampled from the real panel (post hoc), nominal 90% intervals for each configuration's cost and duration cover 63% of the true values on the observed tasks, and their RMS standardised errors are 1.95 and 1.99, against about 1 on datasets simulated from the model's own law. About half of that error is configuration-specific shifts of the interval centre, in both directions, and with those removed the intervals are still 1.4 to 1.5 times too narrow. On held-out real tasks, pooled over five partitions of the tasks, the intervals are modestly too narrow: 87% for completion, 85% for cost and 81% for duration (CYQc follow-up). An attribution test traces the model's lower membership accuracy on the configurations scored to the same source, and the revised analysis reports a task bootstrap alongside the model.
Terminal-Bench v4.1, a regrade released after submission, is a check on the same trials, and all headline numbers stay on v4. GLM-5.3 at C66 is the one configuration whose classification changes, from 0.957 to 0.848 (retained to undetermined).
The revised conclusions reflect these sources: Grok 4.6 and Opus 5 are reported as undetermined rather than as frontier members, each frontier probability names its target, and the trial-level analysis carries cost and duration uncertainty in every draw (revised §5.3 and §6).
Full results are in revised App. E.10 (Table 12 re-estimated), App. E.6 (trial panel and v4.1 check) and App. E.9 (attribution test).