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Under review as a conference paper at ICLR 2027

Candidate-specific Context Coupling for Discrete Diffusion Preference Optimization

Abstract

Preference optimization aligns discrete diffusion models with sequence-level rewards through predictions on partially masked candidates. Existing approaches improve preference objectives and denoising estimates, but uniform masking treats all eligible positions alike. With candidate-specific contexts, the joint sampling of conditional scores also shapes the nonlinear preference objective. We introduce Candidate-specific Context Coupling (), which coordinates reveal progress, counts, and orders while preserving each candidate's selected context distribution. Low-confidence-first supplies a one-pass selector. For fixed Plackett–Luce reveal laws, shared Gumbels simultaneously minimize expected Kendall disagreement on common positions. Under score-response conditions, they also minimize a derived preference-discrepancy upper bound at a fixed joint distribution of shared progress and reveal counts. The method supports pairwise and listwise losses and requires one additional confidence evaluation per candidate. Experiments show gains across DNA sequence design, protein inverse folding, and language modeling, including a 17% relative gain over the strongest baseline in protein inverse folding. Our anonymous code is available at https://anonymous.4open.science/r/C3-C9D7/.

Primary area:
generative models
Keywords:
discrete diffusion models, preference optimization

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.33 over 3 reviews, above 51% of the others.
Reviewer_aiyuOpenReview ↗
Rating
3
Confidence
3
Informativeness
3
Presentation
3
Soundness
3
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Paper summary

This paper proposes C3 (Candidate-specific Context Coupling) for preference optimization of discrete diffusion models. C3 couples the reveal progress, reveal counts, and Gumbel ordering keys across preference candidates while preserving each candidate's marginal distribution over selected contexts, with low-confidence priorities determining which tokens serve as conditioning. The paper proves Kendall-optimal ordering and minimization of a preference-discrepancy upper bound under stated assumptions, and evaluates the method on DNA sequence design, protein inverse folding, and language-model alignment.

Critical strengths
  1. The separation of candidate marginals from their coupling is principled. The shared-Gumbel proof gives compatible full permutations attaining all pairwise Kendall minima, and the loss-bound argument is clearly scoped.
  2. Matched ablations distinguish the priority choice, shared budgets, and shared orders. Fixed-checkpoint loss, variance, and complete-gradient diagnostics provide evidence beyond aggregate generation scores.
  3. The results span three domains and include useful complementary metrics. Protein joint success improves from SDPO's 75.5% to 79.7%, and the paper explicitly reports the accompanying structural trade-off.
Critical weaknesses
  1. Most DNA and protein baseline results are imported from prior work, whereas C3 uses its own training and scoring protocol. In addition, the protein component ablations cover nine epochs while the main result includes two continuation epochs (Appendices C.2 and D.1). These choices complicate attributing the headline improvement to context coupling alone.
  2. Several of the incremental gains need stronger uncertainty analysis. Protein order sharing improves joint success from 77.48 +/- 0.37% to 78.51 +/- 1.04% over three seeds, and the language improvements over the best baselines are small and single-run, including 0.49 points in LC-WR and 0.61 points on HumanEval (Table 3).
  3. The extra completed-candidate confidence evaluation is specified, but its wall-clock and memory overhead are not quantified. Equal-compute comparisons would clarify the practical value of the incremental gains. Moreover, the theory optimizes an upper bound at fixed priorities rather than the actual evolving training objective, so empirical validation remains essential.

The marginal-preserving construction, the sound fixed-priority analysis, and the informative component experiments are valuable; better baseline matching, uncertainty estimates, and cost reporting would strengthen the empirical case.

Questions for authors
  1. How were the baseline training budgets, scoring rules, and selection protocols matched? Do the component gains persist under the full continuation schedule used for the main protein result?
  2. Can you report paired uncertainty for the order-sharing gain, and the stability of the small language gains across training seeds?
  3. What training-time and peak-memory overhead does the confidence pass add, and how do the results compare at equal total compute?
2 comments

Thank you for your careful review and for recognizing the principled coupling construction, the clearly scoped theoretical analysis, and the complementary evidence from component diagnostics and experiments in three domains. Following your suggestions, we have added full-schedule protein controls, paired analyses across training seeds, and training-time and peak-memory measurements.

w1&q1. Imported baselines and protocol differences, together with nine-epoch protein ablations versus the main result’s 9+2 schedule, complicate attribution. How are training budgets, scoring rules, and selection protocols matched, and do component gains persist with continuation?

Thank you for suggesting that we align the ablations with the main training schedule and clarify the scoring and selection protocols. The policy–reference log-probability scores defined in Section 3 are used for preference training, while evaluation follows the same benchmark metrics and success criteria as SDPO (Appendices C.1–C.2). Tables 1–2 identify the imported baseline results, which retain their published training budgets and selection procedures.

To isolate component contributions, all six protein configurations now follow the main result’s 9+2-epoch schedule across three training seeds. They share the same initialization, data, loss, and stage-specific learning-rate and scoring settings, together with the same decoder, sample counts, and evaluation procedure, without reward-based filtering or reranking. Revised Appendix D.1 explicitly states the full schedule and matched settings; updated Table 4 reports the complete results.

Low-confidence selection increases Pred-ddG from 0.858 to 1.644 and Success Rate by 13.22 percentage points over uniform selection, and exceeds high-confidence selection by 28.24 points in Success Rate. Halving the priority strength retains 79.38% Success Rate, close to 79.73% at the default strength. Order sharing alone, with low-confidence selection and the sampling of tt (the expected visible fraction) and visible-token counts unchanged, improves Success Rate by 2.71 points and the fraction with scRMSD < 2 Å by 4.33 points. Full context sharing improves Success Rate by 2.98 points and entropy by 7.68 bits over fully independent contexts. Thus, the gains from low-confidence selection and context coupling persist under the full training schedule.

w2&q2. Small gains need stronger uncertainty analysis: can you report a paired interval for the protein order-sharing gain and test whether the single-run LC-WR and HumanEval improvements persist across training seeds?

We appreciate your suggestion to examine paired uncertainty and the stability of the language gains across training seeds. We have added a paired uncertainty analysis of the full 9+2-epoch results in revised Appendix D.1, Table 4, extending the original nine-epoch comparison cited in your review. This comparison changes only whether the ordering random values are shared, retaining the same low-confidence selection rule and shared sampling of tt and visible-token counts.

MetricPrivate ordersShared ordersPaired gain (points)Paired 95% CI
Success Rate (%) ↑77.02 ± 0.4479.73 ± 0.21+2.71[1.93, 3.50]

The three seed-wise gains are +3.06, +2.44, and +2.64 points: order sharing improves Success Rate in every seed, and its paired interval lies entirely above zero.

For language, we have completed new paired experiments with training seeds 42, 43, and 44 against Diffu-GRPO, the strongest baseline on LC-WR and HumanEval in Table 3. Within each benchmark, both methods use the same generation and scoring settings across seeds. These supplementary evaluations are reported separately from the original single-run Table 3.

Training seedC3 LC-WR (%)Diffu-GRPO LC-WR (%)Gain (points)C3 HumanEval (%)Diffu-GRPO HumanEval (%)Gain (points)
4212.67710.941+1.73650.00045.122+4.878
4312.67212.297+0.37446.95146.9510.000
4412.16711.827+0.33946.95144.512+2.439
Mean ± SD12.505 ± 0.29311.689 ± 0.689+0.81747.967 ± 1.76045.528 ± 1.269+2.439

LC-WR improves in all three training seeds; HumanEval improves in two seeds and ties in one. Their mean gains are 0.817 and 2.439 points, respectively, with paired 95% intervals of [−1.162, 2.796] and [−3.620, 8.498]; both intervals include zero.

± denotes sample SD across training seeds; 95% CIs are paired t-intervals computed from within-seed differences.

w3&q3. Quantify the confidence pass’s wall-clock and peak-memory overhead and compare performance at equal total compute. The fixed-priority upper-bound analysis also needs empirical validation for training with evolving priorities.

Thank you for suggesting a direct assessment of the confidence-pass overhead and performance under a matched training budget. We have measured CUDA-synchronized training-update wall time and peak memory usage. For the single-confidence-pass implementation in Algorithm 1, DNA update time after warm-up increases from 157.3 to 193.2 ms (+22.8%). Peak allocated memory increases by only 0.38 MiB, while peak reserved memory remains 3532 MiB. The confidence pass requires no backpropagation.

Separately, using the main-result continuation implementation, we completed a DNA comparison under a matched training-time budget, allowing the confidence-free control to spend the saved time on additional updates:

MethodUpdatesCumulative update wall time (s)Pred-Activity ↑ATAC-Acc (%) ↑
Uniform, without confidence110–11421.366.330 (0.062)97.97 (0.63)
C35021.216.411 (0.041)98.23 (0.33)

Values are means (sample SDs) across three training seeds. C3 achieves higher mean activity and accessibility even when the control receives more than twice as many updates. The mean gains are 0.081 in Pred-Activity and 0.26 percentage points in ATAC-Acc.

Regarding the theory, training directly optimizes the sampled preference loss, as specified in Algorithm 1. Priorities are recomputed from the current model before each update and held fixed within that update (Section 4.4). Proposition 1 gives an exact conditional ordering guarantee; Corollary 1 connects it to an upper bound on the additional preference loss.

The paper already tests the actual loss and gradient beyond this bound. Section 5.4 and Appendix D.3, Table 6 show that full sharing reduces comparison loss from 0.4328 to 0.3494; order sharing alone reduces it from 0.3607 to 0.3494. Appendix D.5, Table 7 compares complete gradients averaged over 48 context draws with the context-averaged reference gradient: mean cosine similarity across the five candidate collections increases from 0.419 to 0.665, with improvement in every collection. These measurements directly evaluate the preference loss and mean update direction.

Reviewer_VQJ5OpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
1
Soundness
2
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Paper summary

The paper proposes a preference learning algorithm for masked diffusion models, called C3. First, positions are revealed with a preference for low-confidence positions, and candidates in a group are coupled by sharing the same reveal progress and sampling randomness. The theorem proves that shared Gumbels minimize the expected Kendall distance between reveal orders under fixed marginals. Experiments show improvements on protein and language tasks.

Critical strengths
  1. The coupling algorithm is neat and easy to adapt to existing preference learning algorithm and could potentially benefit the broad community.
  2. The experiments show consistent improvement on a series of tasks.
Critical weaknesses
  1. My main concern is that the presentation is hard to follow, making the method difficult to understand. The author mixes the masking heuristic, the coupling design, and the actual algorithm. The main paper repeats abstract terms before explaining the concrete method. For example, in the abstract, “with candidate-specific contexts, the joint sampling of conditional scores also shapes the nonlinear preference objective,” which takes several reads to say that it means independent masks add noise to the score differently. Many terms are used without definition; for example, what are “score-response conditions,” “evidence,” and “reveal progress”? Are these standard terms in preference learning literature or just specific to this paper? There are many open-sentence claims with no intuition or example, such as “Comparison is thus part of context design”. I would suggest a major rewrite of the paper to make it more readable,

  2. The selection rule of this paper, as one major part of the algorithm, is heuristic rather than justified. The ablations provide some empirical support, but the benefits are not consistent across tasks.

Questions for authors

None

3 comments

We thank the reviewer for recognizing the coupling design’s ease of integration into preference learning and C³’s performance gains across tasks. We have clarified the presentation, added matched protein ablations, and examined the DNA selection controls to address the two concerns below.

w1. The presentation mixes the masking heuristic, coupling design, and algorithm. Abstract terms appear before concrete explanations, several terms are undefined, and claims lack intuition or examples.

Thank you for identifying the specific wording and terminology that needed clarification, and for suggesting clearer separation of the selector, coupling design, and algorithm. We have made targeted refinements to the wording and explanations to help readers follow C³’s design and theoretical guarantees more directly.

We now distinguish how each candidate’s context is selected in §4.2, how these contexts are sampled together while preserving each candidate’s context distribution in §4.3, and how the resulting contexts are used to compute the preference loss in §4.4 and Algorithm 1. In particular, the low-confidence choice is explained separately from the coupling guarantee, making the roles of the selector, the coupling construction, and the overall procedure explicit.

In the abstract, we replaced the compressed sentence highlighted in the review with a direct explanation: independently sampled masks can make candidate comparisons depend on which tokens happen to be visible. The abstract and introduction then describe the method through its concrete operations—prioritizing low-confidence positions and sharing the randomness controlling visible-token counts and reveal orders.

We have also clarified the terms raised in the review. “Reveal progress” was shorthand for tt, which §3 now defines as the expected visible fraction among positions considered for masking. “Score-response conditions” referred to bounds on score changes when visible positions change at the same tt and visible count; §4.3 now states this assumption directly. The informal “evidence” wording in the main text has been replaced by “candidate scores,” defined in §3. These labels were explanatory shorthand in our exposition; “evidence lower bound” retains its standard meaning.

The introduction uses subject–verb examples linked to Figure 1 to explain why visible content matters both within a candidate and across candidates. Section 4.1 also unpacks the statement about comparison and context design: coupling determines which candidate scores occur together, so a nonlinear preference loss can have different expectations even when the individual score distributions are unchanged.

w2. Low-confidence selection is heuristic rather than sufficiently justified, and the ablations show inconsistent benefits across tasks.

Thank you for highlighting the need to explain the low-confidence choice and examine whether its benefits extend across tasks. Our ablations show gains from low-confidence selection in both protein and DNA design. The rule is motivated by the role of visible tokens as context: revealing a candidate’s own token at a position where the model is less confident makes that content available for predicting the remaining tokens under sequence-level reward supervision (§4.2). To evaluate this choice directly, we hold context coupling fixed and compare low-confidence, uniform, and high-confidence selection.

For protein inverse folding, the matched three-seed ablations in updated Appendix D.1, Table 4 show that low-confidence selection improves median Pred-ddG from 0.858 to 1.644 and Success Rate from 66.5% to 79.7% compared with uniform selection. Reversing the priority direction to favor high-confidence positions gives 51.5% Success Rate, so low-confidence selection yields a 28.2-percentage-point improvement over this reversed rule.

For DNA design, Appendix D.2, Table 5 evaluates the selection rule with the same aligned coupling. Relative to uniform selection, low-confidence selection improves 3-mer correlation from 0.886 to 0.911, JASPAR correlation from 0.942 to 0.956, and positional entropy from 352 to 356 bits. All three improvements occur in each of the three training seeds. Thus, the selection rule benefits both tasks through higher predicted stability and joint success for proteins, and better sequence-statistic agreement and diversity for DNA.

Thank the author for their reply. The response does not fully address my concern. Improving the presentation would require a significant revision. Therefore, I tend to keep the current score.

Thank you for the follow-up. We have revised the exposition throughout the abstract, introduction, preliminaries, and method section, while keeping the underlying method unchanged. We would appreciate your assessment of these revised passages. If a specific step or passage remains unclear, could you point it out so that we can address it directly?

Reviewer_LK1WOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
1
Soundness
3
Read review
Paper summary

The authors propose C3 for coupling candidate-specific contexts in nonlinear preference learning. The proposed method improves DNA design, protein inverse folding and language modeling.

Critical strengths

The coupling idea is clean and cheap: sharing random keys changes only the joint distribution while provably preserving each candidate’s context marginal, so the method costs one detached forward pass plus a sort per candidate and drops into existing pairwise or listwise objectives. So the method is fairly efficient.

Critical weaknesses

The experimental improvements obtained by the method are not groundbreaking. Very often, C3 is better than baselines in some metric, yet worse in another:

  1. The headline “17% protein gain” is on Pred-ddG, the optimized reward, while scRMSD actually worsens (0.938 -> 1.063) and structural success drops 2.5 points versus SDPO, so joint success rises mainly by trading structure for reward.
  2. DNA gains over SDPO are within or near a seed standard deviation (6.30 -> 6.41), and key-correspondence effects (6.406 vs. 6.367) are smaller than the reported SDs.

The ablation studies show that the largest drop comes from progress sharing, while the contribution of the paper (the order alignment) only improves it by 3.1%.
This may be due to gaps between theory and eperiment:

  1. The theory only minimizes an upper bound with unestimated constants (L_j, V_ij).
  2. The bound only holds for frozen priorities.
Questions for authors

To what extent do the theoretical guarantees apply to the experiments? To what extent does the main technical novelty actually improve the quantitative performance? Do you see ways to improve some metric without deteriorating others (and thereby not merely moving along some pareto front)?

2 comments

Thank you for recognizing that C3 preserves each candidate’s context distribution while remaining efficient to apply. We clarify how the existing theory connects coupling to preference loss, and present ablations over the full training schedule and a comparison with official SDPO to quantify component gains and reward–success trade-offs.

w1a. The 17% gain is on the optimized reward; joint success mainly rises by trading structure for reward.

The 17.4% gain refers specifically to Pred-ddG, as reported in Table 2. We have made the metric name explicit in the abstract and introduction. Our post-training preferences use the benchmark’s stability reward; the backbone remains the conditioning input, while structural consistency is evaluated separately. Stability therefore receives direct supervision, and structural metrics need not improve simultaneously. Table 2 reports higher Pred-ddG and an increase in joint success from 75.5% to 79.7%, alongside a decrease of 2.5 percentage points in structural success. We accept this measured trade-off because, under unchanged success criteria, C3 produces a larger fraction of candidates that are both predicted-stable and backbone-consistent. If simultaneous improvement in structural metrics is required, incorporating a structure-aware reward could provide a direct optimization signal. Here, we retain the benchmark reward to evaluate our method without introducing an additional reward-design change.

w1b. DNA gains over SDPO are within or near a seed SD; key-correspondence effects are smaller than the reported SDs.

In Table 1, C3 achieves 6.41 ± 0.020 Pred-Activity, compared with 6.30 ± 0.003 for SDPO. The mean difference of approximately 0.11 is 5.5 times the larger reported SD. C3 also improves accessibility (94.8%→97.7%), 3-mer correlation (0.900→0.911), and JASPAR motif correlation (0.936→0.956). Table 5 isolates the key-correspondence effects by comparing shared and independently sampled Gumbel ordering keys. Sharing these keys yields an observed mean activity gain of 0.0384, with positive paired differences in two of three training seeds. Shared ordering keys improve the mean activity of generated DNA, demonstrating their practical contribution to the design objective. Appendix D.2 explicitly defines these controls. The paired differences below are a reanalysis of the existing Table 5 experiments.

Activity difference: shared − independent ordering keysSeed 0Seed 1Seed 2Mean
Pred-Activity−0.0055+0.0630+0.0576+0.0384

w2. Progress sharing gives the largest ablation drop, while order alignment—the claimed core contribution—adds only 3.1%.

Thank you for analyzing the contributions of progress sharing and order alignment, and their connection to the theoretical guarantees. Here, “progress sharing” means using a common tt, the expected fraction of eligible positions that are visible. It is an integral part of C3’s construction, which coordinates tt, visible-token counts, and candidate-specific reveal orders. The 3.1% in Section 5.4 and Appendix D.3, Table 6 is an additional reduction in comparison loss at a fixed model and batch, after tt and visible-token counts are already shared. Appendix D.1, Table 4 evaluates the contribution of order sharing to final generation under the full 9+2-epoch schedule. Comparing Low/private orders with Low/full (−7.5), sharing ordering keys increases Success Rate by 2.71 percentage points and structural success by 4.33 points, with both gains occurring in all three training seeds. These results quantify the downstream contribution of order alignment beyond the fixed-model loss diagnostic.

w2a. The theory only minimizes an upper bound with unestimated constants.

Our theory directly targets the additional preference loss caused by context sampling. Proposition 1 in Section 4.3 proves that shared Gumbels minimize the expected Kendall distance simultaneously for every candidate pair, while preserving each candidate’s Plackett–Luce distribution over complete reveal orders. Kendall distance counts position pairs ordered differently in the two reveal orders. This result involves neither LjL_j nor VijV_{ij}. Corollary 1 then connects this ordering guarantee to an upper bound on the additional preference loss ΔΠ\Delta_\Pi. When comparing order couplings, the constants remain fixed, and every term of the bound is nondecreasing in its corresponding expected disagreement. Shared Gumbels minimize all these disagreements simultaneously, so they minimize the bound for every admissible choice of the constants. Their values determine the bound’s numerical size and tightness, but are unnecessary for selecting this coupling. These two guarantees were already stated in Proposition 1 and Corollary 1. We have clarified how the exact ordering result leads to minimization of the derived bound on this additional loss.

w2b. The bound only holds for frozen priorities.

“Frozen priorities” means fixed within an optimizer update, not throughout training. In Algorithm 1, the current policy first evaluates each completed candidate once to compute confidence and reveal priorities. These priorities are computed without gradients and held fixed while fresh contexts are sampled and the preference-loss gradient is computed. The next update recomputes them using the updated policy. Conditioning on the current training history and priorities therefore gives the fixed-priority setting required by the analysis. The marginal-preservation and ordering-optimality guarantees apply conditionally at each sampling step, and the preference-loss bound applies under its stated assumptions. Section 4.4 and Appendices B.1–B.2 explicitly state this existing per-update rule. We have expanded Algorithm 1 to make the existing computation order explicit and avoid interpreting “frozen” as fixed throughout training.

q1. To what extent do the theoretical guarantees apply to the experiments?

Section 4.1 decomposes the expected preference loss into a context-averaged reference and an additional term introduced by applying the nonlinear loss to sampled candidate scores. With the model and candidate group fixed, preserving each candidate’s score distribution keeps the reference unchanged, so the measured loss decrease equals the decrease in this additional term. The diagnostics already reported in Section 5.4 and Appendices D.4–D.5 examine this relationship. In all eight groups with identical empirical score marginals, coupling lowers preference loss and reduces the variance of differences between candidate scores by 94.67–98.14%. Appendix D.5, Table 7 additionally compares the gradient of the sampled preference loss, including all candidates’ contributions, with the gradient obtained by averaging candidate scores across contexts before applying the same loss. Full coupling increases the mean cosine similarity from 0.419 to 0.665, with improvements in all five evaluated candidate collections. These results show that coupling reduces this additional preference loss and makes sampled gradients better aligned, on average, with the context-averaged reference gradient.

q2. To what extent does the main technical novelty actually improve the quantitative performance?

C3 selects context within each candidate and coordinates context sampling across candidates. In our new full-schedule protein experiments (updated Appendix D.1, Table 4), low-confidence selection raises Pred-ddG from 0.858 to 1.644 and joint success from 66.51% to 79.73% compared with uniform selection. With the selection rule and shared sampling of the expected visible fraction tt and visible-token counts unchanged, order sharing alone improves joint success by 2.71 percentage points and structural success by 4.33 points. With the low-confidence-first selection rule unchanged, full context sharing improves joint success by 2.98 percentage points and entropy by 7.68 bits over fully independent contexts. For DNA, Appendix D.2, Table 5 already reports that, with coupling fixed, low-confidence selection improves 3-mer correlation from 0.886 to 0.911, JASPAR motif correlation from 0.942 to 0.956, and entropy by 4.18 bits over uniform selection. All three DNA improvements occur in every training seed. With the low-confidence-first selection rule unchanged, aligned ordering keys further increase mean activity from 6.367 to 6.406. These controls quantify contributions from both context selection and coupling.

q3. Do you see ways to improve some metric without deteriorating others (and thereby not merely moving along some pareto front)?

Yes. Table 1 already shows that C3 outperforms the strongest compared baselines in DNA activity, accessibility, and JASPAR motif correlation. Table 3 reports the best AlpacaEval WR/LC-WR, HumanEval, and MBPP scores; C3 also improves all six reported language metrics over both SDPO and diffu-GRPO. For protein design, Appendix D.7, Figure 6 (newly added) compares the Pred-ddG–joint-success trade-off against official SDPO. C3 achieves 1.617 Pred-ddG with 78.78% joint success, and 2.240 with 77.67%. Both configurations exceed the highest SDPO Pred-ddG (1.462) and highest SDPO joint success (77.21%) in the plotted comparison. The benefit goes beyond trading structure for higher Pred-ddG: under unchanged structural criteria, C3 produces a larger fraction of candidates that are both predicted-stable and backbone-consistent. These simultaneous gains improve upon the entire observed SDPO frontier, rather than merely moving along it.

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