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Under review as a conference paper at ICLR 2027

SciEvoBench: Forecasting Scientific Method Transitions from Historical Evidence

Abstract

Scientific progress is shaped by how new methods build on and change existing ones. Recent benchmarks evaluate large language models (LLMs) on forecasting future scientific contributions, but predicting a contribution alone does not make explicit how an existing method develops into a successor. We introduce SciEvoBench, a benchmark for method transition forecasting built on SciEvoEnv, a two-layer graph environment linking papers, extracted methods, and their evolution relations. Given a source method and the scientific record available at a specified time, the Event task predicts whether a successor will first be observed within three months. For realized events, the Content task predicts the affected source aspect (Where) and successor mechanism (What). Both tasks support Static evaluation from fixed evidence and Dynamic evaluation through interactive exploration. Evaluations of open-weight and proprietary models show that Dynamic access improves Event discrimination for some models, while identifying potential improvement directions remains easier than predicting successor mechanisms. Structural baselines reveal predictive signal in relations and recency beyond activity alone. Controlled analyses with Qwen3.5-9B show that Dynamic forecasts match more recorded mechanisms without a reliable increase in target-window matches. Early reading mainly improves valid-answer coverage; further reading, re-answering, and evidence replacement yield no reliable gain in mechanism prediction. These findings distinguish access to predictive information and related knowledge from anticipating a specific technical change at the right time.

Primary area:
datasets and benchmarks
Keywords:
Scientific forecasting, science of science, scientific method evolution, large language model, graph reasoning, benchmark evaluation

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_CdkWOpenReview ↗
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3(+1)
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3
Informativeness
2
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Soundness
1
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Paper summary

This paper introduces SciEvoBench, a benchmark for forecasting how existing scientific methods evolve into successors. It is built on SciEvoEnv, a two-layer graph environment constructed from about 1.13 million computer-science works, which links papers and their citations to extracted method identities and their dated lineage and substitution transitions. Given a source method and the evidence available up to a cutoff time, the Event task predicts whether a new successor will first appear within the next three months, and the Content task predicts which aspect of the source method changes and what mechanism the successor introduces. Both tasks are evaluated in a Static mode with fixed evidence and a Dynamic mode with bounded interactive exploration of the graph. Experiments on 1,695 matched pairs with open-weight and proprietary models show that interactive access improves event discrimination for only some models, and that identifying the affected aspect is consistently easier than predicting the specific mechanism. Structural baselines show that graph relations and recency carry predictive signal beyond publication activity, while controlled analyses show that additional evidence, re-answering, or evidence gathered by stronger agents does not reliably improve mechanism prediction.

Critical strengths
  1. The paper addresses a frontier and valuable research question, asking whether LLMs can anticipate how existing scientific methods evolve into new ones. Framing forecasting around concrete method transitions offers a finer-grained and more interpretable target than prior work on predicting topics or contributions.

  2. The work is built on a large-scale and carefully processed data foundation, covering over one million computer-science works linked to persistent method identities and dated evolution relations. The environment is well documented and can serve as a reusable resource for studying method evolution.

  3. The evaluation design and analyses provide meaningful insight beyond leaderboard numbers. By comparing fixed-evidence and interactive settings under the same historical cutoff, the paper shows that more access to evidence helps models reproduce recent mechanisms but not anticipate the specific change that actually occurs, revealing a clear gap between retrieving knowledge and forecasting scientific progress.

Critical weaknesses
  1. The evolution relations capture what authors claim in titles and abstracts rather than actual methodological derivation. The paper does not discuss the validity of this proxy, including how authors' self-positioning and the omission of predecessors mentioned only in the full text may bias both positive and negative labels.

  2. The Event target is defined as the first observation of a successor in the corpus, which depends on publication and release timing rather than when a methodological change actually occurs. The paper does not discuss this gap between observation and development, nor quantify how much release timing contributes to the labels within such a short window.

  3. The reliability of the evaluation targets is unresolved. The construction audit supports the evolution class with all grounding checks for only about 31% of sampled edges, yet the labels remain unchanged and no analysis shows whether the main findings hold on verified targets.

  4. Human oversight is very limited. The construction audit and the judge validation each rely on a single human reviewer covering about fifty cases, and the mechanism-matching and intervention analyses receive no human validation at all.

  5. The paper does not examine two assumptions behind its labels. Negative labels treat missing edges as the absence of a successor, although they lie outside the audit. Each three-month Content task has a single reference, although a method can plausibly evolve in several directions, so low mechanism scores may partly reflect task underdetermination rather than model inability.

Questions for authors
  1. Do the main findings hold on a verified subset of evaluation targets, given the disagreements found in the construction audit?

  2. To what extent do the recorded evolution relations reflect actual derivation rather than how authors position their work in abstracts, and how might this bias negative labels?

  3. How sensitive are the Event labels to publication timing and to whether input text was truly available before each cutoff?

  4. Since each Content task has a single reference while a method may evolve in several plausible directions, how should the low mechanism scores be interpreted?

5 comments
AuthorsOpenReview ↗

Response to Reviewer CdkW (1/2)

Thank you for recognizing the dataset’s value and the distinction we draw between retrieving a known mechanism and forecasting when it will emerge. Our responses are as follows:

Q1: Do the main findings hold on a verified subset of evaluation targets?

A1: Thank you for suggesting this check. We used common-600, the stratified sample of 600 matched Event pairs (of 1,695) used for cross-model comparisons (Appendix D). Each positive also supplies a Content task. In the cross-model evaluation, one subset required support for the positive from at least two of Qwen, GPT-6.1-Sol and DeepSeek. The other required both GPT-6.1-Sol and DeepSeek. For Event, we excluded pairs if a retrieved candidate for the negative met the same rule. In the expanded human review, annotators checked a stratified sample of 72 positives against their papers and retained 57 for Content. Our response to Reviewer 7ef4, Q1 gives details.

With forecasts and scores fixed, the main findings held on the verified subsets (Table 1, column headings give Content targets / Event pairs). The two significant Dynamic Event AP gains in §4.2 (Qwen3.8-27B and Gemini) stayed positive on both model-verified subsets, though only one of the four 95% intervals excluded zero. Where still scored above What (§4.3). Graph relations significantly improved Event AP over publication activity on both model-verified subsets (§5.1). Qwen3.5-9B’s Dynamic forecasts matched more recorded mechanisms overall, with no clear gain within the forecast window (§5.2). We will report these comparisons alongside the original results in §§4–5.

Table 1. Main findings on verified subsets.

FindingFull (600 / 600)≥2 verifiers (378 / 205)GPT and DeepSeek (203 / 143)Human review (57 / —)
Dynamic − Static Event AP, Qwen3.8-27B / Gemini (§4.2)+0.044 / +0.033+0.088 / +0.031+0.023 / +0.035—
Where > What, models with 95% CI above zero, Static / Dynamic (§4.3)8/8 / 7/88/8 / 7/88/8 / 7/88/8 / 7/8
Mean Static What (§4.3)1.171.181.171.15
Event AP gain from adding graph relations to publication activity (§5.1)+0.093+0.082+0.097—
Qwen3.5-9B Dynamic − Static mechanism match rate, any date / in-window (§5.2)+0.071 / −0.004+0.064 / −0.003+0.048 / −0.012+0.098 / +0.039 (51 tasks, 3 Dynamic vs. 1 Static in-window matches)

Q2: To what extent do the recorded evolution relations reflect actual derivation rather than how authors position their work in abstracts, and how might this bias negative labels?

A2: Thank you for raising this question. To record a transition, the extractor must quote a passage from the abstract describing how the new method changes a named predecessor (Appendix C.4–C.5). Application, component use or citation alone is insufficient. Each link captures the change the authors report. We checked whether papers supported these links and whether missed links produced false Event negatives.

Human review. For the 72 positives in Q1, annotators judged 62 links decidable from the abstract alone and consulted the introduction for the other ten. They agreed with the recorded evolution in 71/72 cases and with the link between the named methods in 60/72 (83.3%, including partial identity support). Abstracts thus usually sufficed to judge the derivation, and the review supported most recorded links.

Missed successors. The graph can miss a predecessor link described only in the body. To check the effect on Event labels, we reviewed 49 negatives, oversampling machine-flagged ones, and found in-window successors for 28. Weighted to all 600 negatives, this corresponds to 39–48%. In 26 cases, the successor paper was already in the corpus. After correcting all 28 labels, the Dynamic and graph-feature AP gains remained positive (§§4.2, 5.1, see our response to Reviewer qkve, Q2).

A missed successor can also leave a Content forecast without a matching reference. We therefore searched each window by source name, alias and citations, took each task’s top eight corpus hits besides its reference, and added web search for 30 tasks. For 314 of 600 tasks, GPT-6.1-Sol found a passage in another paper documenting a change to the source method. Q4 measures the effect on Content scores.

Re-extraction with body excerpts. We collected 600 full texts and reran Qwen3.8-27B on 599 with a distinct introduction (Appendix C.2). GPT-6.1-Sol judged both outputs against the same passages, blind to condition. On 598 papers judged twice, it rated 74.7% of extractions faithful with body excerpts and 65.0% with abstracts alone. In both orders it preferred the body-augmented output for 153 papers. The abstract-only output was still better for 86, likely because the longer context made the change harder for the 27B extractor to find. We will clarify the scope of the links in §3.1 and report this test in Appendix C.

AuthorsOpenReview ↗

Response to Reviewer CdkW (2/2)

Q3: How sensitive are the Event labels to publication timing and to whether input text was truly available before each cutoff?

A3: Thank you for raising both the timing of the event and the evidence available to the forecaster.

First public disclosure. The Event task forecasts when a successor to the source method is first publicly documented in our corpus, within the three-month forecast window (§3.2, Eq. 1). Development may begin earlier, but first disclosure is the earliest dated public record a label can verify. We date each successor by its earliest public record, which fell within the assigned window for all 600 positive targets in common-600. Release timing still matters. Of these papers, 43 had both a preprint and a linked conference record, and using the conference year alone would place all 43 after their windows.

Availability of historical inputs. We checked the frozen abstracts in the Static inputs for later revisions (Appendix C.1). Abstracts appeared 18,530 times across the 1,800 common-600 Static prompts. For 15,253 occurrences, we retrieved the arXiv abstract available at the cutoff. GPT-6.1-Sol flagged 528 of the checked occurrences (3.5%) for added technical details, revised results or an apparent paper mismatch, indicating possible exposure to later information (see our response to Reviewer qkve, Q3).

We excluded a Content target if its Static input cited a flagged paper and an Event pair if either member did. On the 375 retained Event pairs, the Dynamic AP gains reported in §4.2 remained positive for Qwen3.8-27B (+0.036) and Gemini (+0.028), although both 95% intervals included zero. On the 452 retained Content tasks, mean Static What stayed at 1.17 and Where remained significantly higher than What for all eight models in Static and seven in Dynamic (§4.3). We will clarify the label date in §3.2 and report the results after excluding affected inputs.

Q4: Since a method may evolve in several plausible directions, how should the low What scores against a single reference be interpreted?

A4: Thank you for pointing this out. A single reference can give too little credit to a forecast that matches another successor observed in the same window. We therefore rescored the original forecasts with additional references, keeping the judge and rubric fixed (Appendix F.1).

Reference expansion. From the Q2 search, we added 721 model-verified references across 314 of the 600 Content tasks after deduplication and a cap of five per task. For ten tasks with candidates, we checked the alternatives against their papers and first public dates. Human review confirmed 16 in-window successors across nine tasks.

What the additional references captured. Mean What rose from 1.20 to 1.55 on the 314 tasks and from 1.18 to 1.63 on the nine with human-confirmed alternatives. Of 5,024 outputs (314 tasks × eight models × two modes), 1,426 gained points. Of these, 892 moved from 1 to 2 (a shared goal or broad approach) and 393 from 1 to 3 (part of the realized technical operation). The judge selected an added reference in 1,087 of these 1,285 cases.

The number scoring 4 or 5 on What rose from 33 to 83 (1.7% of outputs). Single-reference scoring thus missed some partial matches. Even with expanded references, few forecasts identified the defining operation of an observed successor (§4.3). We will release the additional references with their supporting papers and identify those confirmed by human review.

Additional concern (W4). Human oversight. Thank you for highlighting the limited human coverage. We expanded the target and Content-judge audits and added human checks of the mechanism matches (§5.2) and evidence interventions (§5.3). Table 2 gives the sample size for each check and the number independently reviewed by both annotators. We will add the human review results and scoring criteria to the appendix.

Table 2. Human review.

ModuleReviewed / overlapFinding
Positive targets72 / 20Agreement on Content retention in 16/20 shared cases.
Event negatives49 / 20Agreement on a qualifying successor in 17/20 shared cases.
Content judge (Appendix F.2)40 answers / 40Both annotators and the LLM judge scored Where above What on the same answers.
Mechanism matches (Appendix M)10 / 5One annotator confirmed 3 exact and 6 partial matches. The other confirmed matches in all 5 shared cases.
Evidence replacement (Appendix N.2)10 pairs / 5With evidence from another agent or a retrieval rule, the human What score stayed the same in nine of ten pairs and fell in one.

Presentation. In §§4–5, we will state the question each analysis addresses and explain how its results support the conclusion. In the appendix, we will clarify how we construct the benchmark and evaluate forecasts. Thank you again for your detailed comments, and we are happy to answer any further questions.

Dear Reviewer CdkW,

Thank you sincerely for your time and effort. With ICLR receiving a record number of submissions this year, we know the workload on reviewers is especially heavy, and we truly appreciate your careful review.

As the reviewers currently hold differing views on our paper and the discussion period closes tomorrow (November 18), we would greatly value your further thoughts. In our November 13 response and revised PDF, we addressed each of your points --- specifically verifying our main findings across model- and human-validated subsets, auditing abstract-only extraction against full texts and missed successors, checking cutoff timing and revised arXiv inputs, expanding Content evaluation to multi-reference targets, and broadening our human audits across modules.

If any concerns remain, even a brief line would be hugely helpful, and we will gladly respond before the deadline.

Best regards,
The Authors

Reviewer_qkveOpenReview ↗
Rating
3(+1)
Confidence
3
Informativeness
2
Presentation
3
Soundness
1
Read review
Paper summary

This submission proposes SciEvoBench, a benchmark for scientific method transition forecasting, based on SciEvoEnv, a graph environment linking papers, extracted methods, and their evolution relations. Given a source method and the scientific record available at a specified time, the Event task predicts whether a successor will first be observed within three months. Conditional on a realised event, the Content task predicts the affected source aspect (Where) and successor mechanism (What). Both tasks support Static evaluation from fixed evidence and Dynamic evaluation through interactive exploration. Results show that Dynamic access improves Event discrimination for some models, while identifying potential improvement directions remains easier than predicting successor mechanisms.

Critical strengths
  1. The idea of decomposing scientific research contribution into successor emergence and where and what of technical changes is reasonable, and makes evaluation actionable.
  2. The proposed evidence-method scientific environment enables th comparison of inference from evidence or iterative evidence acquisition.
Critical weaknesses
  1. The construction primarily relies on LLM annotation, while the human panel comprises only 50 cases judged by one reviewer, including 15 evolution cases; 5 of these are classified as application, component use, or noise. When using an LLM (GPT-5.5) as a cross-annotator, the evolution class and all 5 checks reach only 30.6% weighted support. These results reveal substantial annotation uncertainty and quality.

  2. Missing papers, extracting at most one main contribution, and failures in identity resolution or relation adjudication can leave transitions unrecorded. I see that Appendix C.6 explicitly excludes missing edges and negative benchmark labels. Thus, no recorded successor need not mean that no qualifying successor occurred. The graph-wide analysis partially addresses alternative support, but is not exhaustive graph-wide semantic adjudication and does not repair the labels. These omissions can create false negatives in Event and penalise Content forecasts that match actual but unrecorded developments.

  3. A question about the setting is that the submission uses arXiv and conference versions and filters historical evidence. Although it acknowledges that revision-level text availability is not guaranteed, some evaluation windows also precede a model's documented knowledge cutoff, while authoritative cutoff dates remain unverified for several models. Thus, the evaluation cannot fully distinguish forecasting from recalling subsequently published developments.

Questions for authors

Please see above.

5 comments
AuthorsOpenReview ↗

Response to Reviewer qkve (1/2)

Thank you for highlighting the distinction between Event and Content and our comparison of fixed evidence with iterative retrieval in the same environment. Our responses are as follows:

Q1: The construction relies on LLM annotation. The human panel has 50 cases from one reviewer, 5 of 15 evolution cases are application, component use or noise, and the GPT-5.5 cross-check reaches 30.6% joint support.

A1: Thank you for highlighting the limited human review and the disagreement in the construction audit. The 30.6% in Appendix C.6 is the weighted share of audited edges for which GPT-5.5 supported both the evolution class and all five grounding checks (endpoints, direction, technical change, Where and What). Edges with insufficient evidence for any check remain in the denominator.

Disagreements in the construction audit. We used GPT-6.1-Sol to classify GPT-5.5’s reasons for rejection (Table 1, unweighted counts with percentages weighted by stratum as in Appendix C.6). Only edges meeting Eq. 1, where the successor’s first paper documents its relation to the named source within the window, can become Event targets. Of 179 edges, 72 qualified. GPT-5.5 retained 51, left 12 unresolved and rejected nine, including five where it judged the relation unsupported. Of the 33 edges rejected over method specificity, 30 were ineligible. Specificity disagreements therefore rarely define evaluation targets, although they remain in the graph that forecasters can query. For eligible edges, the main risk is a wrong method identity, which the expanded review below measures.

Table 1. GPT-5.5 audit judgments.

Audit judgmentEvolution edgesIdentity merges
Retained92/179 (50.8%)79/182 (43.3%)
Unresolved3234
Rejected over method specificity3364
Rejected because the relation or identity fails215
Other rejection10

The original human review. The annotator judged five of 15 edges to be non-evolution cases. Three were ineligible as Event targets because the graph merged a new method into one it used (e.g., an MRI sampling method into the straight-through estimator). Both errors among the seven eligible edges concerned method identity. We therefore checked both method identities in our new sample.

Expanded human review. We sampled 72 positive evaluation targets by stratum from common-600 (Appendix D). One annotator reviewed all 72 and another independently reviewed 20. They agreed on evolution in 20/20 and on Content retention in 16/20 (κ = 0.57). The papers supported the transition and both method identities in 60/72 cases (including partial identity support). Both Where and What aligned with the paper in 63/72.

On the 57 retained Content targets, Where still scored significantly above What for all eight models in Static and seven in Dynamic (§4.3). On both model-verified Event subsets, adding graph relations to publication activity still improved AP (§5.1, see our response to Reviewer 7ef4, Q1). We will report the audit breakdown and expanded review in Appendix C.6.

Q2: Missing papers, single main contributions and identity or relation failures can leave transitions unrecorded, creating Event false negatives and penalizing Content forecasts.

A2: Thank you for raising this point. We estimated how often negatives miss a successor, measured the effect on both tasks and repaired the affected negatives.

Finding missed successors. For each of the 600 negatives, we retrieved in-window papers by source-method name, alias and citation. The top 32 recovered 609/768 known successors on held-out positives. GPT-6.1-Sol checked for a quoted change to the source with an identifiable Where and What. We flagged 261/600 negatives (43.5%) for which GPT-6.1-Sol and at least one of Qwen and DeepSeek supported the same candidate. A web search with Codex CLI (GPT-6.1-Sol) on 100 negatives (50 per group) found model-supported candidates outside the retrieved list for 39. The rates below thus cover only omissions visible to in-corpus retrieval. We reuse this search to audit the replacement negatives.

Human review. To check for both false alarms and misses, annotators reviewed candidates from both groups, blinded to group and machine verdict (Table 2). They agreed on 17/20 shared negatives (κ = 0.66). Weighting the two groups by their shares among the 600 negatives gives a missed successor for 39% under full source-identity support, or 48% including partial support. In 26 of the 28 human-confirmed omissions, the successor paper was already in the corpus. Its missing link to the source method produced the false negative.

Table 2. Negatives with human-confirmed successors.

Sampling groupFull source-identity supportFull or partial support
Flagged (34 reviewed)19/3423/34
Unflagged (15 reviewed)4/155/15
AuthorsOpenReview ↗

Response to Reviewer qkve (2/2)

A2 (continued). Effect on Event findings. With forecasts fixed, the Dynamic AP gains for Qwen3.8-27B and Gemini remained positive after we corrected the 28 confirmed omissions (§4.2, Table 3 in our response to Reviewer 7ef4). Table 3 below tests how further corrections affect the AP gain from adding graph features to publication history (§5.1).

Table 3. Graph-feature AP gain under label corrections.

Event labelsEvent setAP gain
Original labelsfull+0.064
28 confirmed omissions relabelled positivefull+0.062
Original labelscommon-600+0.093
Reviewed labels fixed, other negatives relabelled at the review rates (68% of flagged, 33% of unflagged, 500 draws)common-600+0.043 [0.019, 0.067]
Hypothetical stress test relabelling the 737 lowest-scoring negatives under the graph-only model (43.5% of 1,695)full−0.108

Correcting the confirmed omissions barely changed the full-set gain. Further corrections at the human-review rates roughly halved the common-600 gain, which stayed positive. Concentrating changes among the lowest-scoring negatives reversed it.

Effect on Content forecasts. For 314 of the 600 targets, our search found additional model-verified in-window successors. Adding these references with forecasts and judge fixed raised mean What from 1.20 to 1.55 on those tasks. Even with the additions, only 83 of 5,024 outputs scored 4 or 5 on What, and Where still scored higher (§4.3, see our response to Reviewer CdkW, Q4).

Repairing the negative labels. We kept each flagged pair’s positive and sought a matched negative with no verifier-supported successor among its top 32 candidates. Exact matching supplied 180 replacements. Close matches on activity and branch count added 76. Together with the 339 unflagged pairs, the resulting 595 pairs remained balanced on visibility, activity, age and branch count (absolute standardized differences ≤0.01). The web search then found possible successors for 33 of the replacements. Table 4 scores both sets against the same 595 positives, one run per model.

AP rose for GPT-5.5 (+0.024), Qwen3.8-27B and Qwen3.5-9B, and changed little for the others, including Gemini. The replaced negatives thus included successors that stronger forecasters ranked high. The six open models kept their order, so the model comparisons in §4.2 are unchanged. Both findings held on the 519 exact-match pairs and after excluding the 33 web-flagged replacements or five unflagged negatives with human-confirmed successors (Table 2).

Table 4. Static Event AP before and after repair.

ModelOriginal negativesUpdated negatives
Qwen3.8-27B0.5820.597
Qwen3.5-9B0.5580.578
Qwen3-8B0.5300.529
Qwen3-4B0.4950.498
Llama-3.1-8B0.5030.505
Llama-3.2-3B0.4880.494
GPT-5.50.5790.603
Gemini-3.8-Flash0.5810.582

We will apply this screening to every Event negative, release the repaired labels as the official version, report the main tables on them and document per-target decisions in Appendix C.6.

Q3: The submission uses arXiv and conference versions, revision-level text availability is not guaranteed, and some windows precede a model's documented cutoff.

A3: Thank you for raising these questions about timing and prior exposure.

arXiv and conference dates. We use the earlier public date (Appendix C.1). All 600 audited targets fell within their windows (see our response to Reviewer CdkW, Q3 for the conference-date comparison).

Abstract revisions. Both modes use frozen abstracts. In 1,200 Event and 600 Content Static prompts, abstracts appeared 18,530 times. We retrieved the cutoff-date arXiv version for 15,253 occurrences. GPT-6.1-Sol flagged 528 (3.5% of those checked) for added technical content, revised results or a paper mismatch, indicating possible post-cutoff exposure.

We excluded Content targets whose Static input cited a flagged paper and Event pairs if either member did. On the remaining 452 targets, mean Static What stayed at 1.17 and Where remained significantly above What for 8/8 models in Static and 7/8 in Dynamic (§4.3). On the remaining 375 pairs, Dynamic AP gains for Qwen3.8-27B and Gemini stayed positive, though both 95% intervals included zero (§4.2).

Model cutoffs. We used the documented cutoff or, for open models without one, the weight release. After the boundary, Event AUROC fell in all six Static comparisons and moved in both directions in Dynamic. Changes in mean What ranged from −0.10 to +0.09 points. Tasks differ across periods, limiting inference about prior exposure (see our response to Reviewer 7ef4, Q2, Table 4).

We will add the revision breakdown to Appendix C.1 and the model-cutoff comparisons to Appendix L. Thank you again for your comments, and we are happy to answer any further questions and engage in discussions.

Dear Reviewer qkve,

Thank you sincerely for your time and effort. With ICLR receiving a record number of submissions this year, we know the workload on reviewers is especially heavy, and we truly appreciate your careful review.

As the reviewers currently hold differing views on our paper and the discussion period closes tomorrow (November 18), we would greatly value your further thoughts. In our November 13 response and revised PDF, we addressed each of your points --- specifically breaking down the GPT-5.5 construction audit alongside an expanded dual-annotator review, quantifying missed successors and repairing the affected Event negatives (with updated model results), and verifying robustness across cutoff-date arXiv revisions and pre-/post-cutoff splits.

If any concerns remain, even a brief line would be hugely helpful, and we will gladly respond before the deadline.

Best regards,
The Authors

Reviewer_7ef4OpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

SciEvoBench studies whether LLMs can forecast how an existing scientific method will develop into a successor. The authors build SciEvoEnv from papers, extracted methods, and their evolution relations. The benchmark predicts whether a successor will appear within the next three months, and, if so, which part of the original method will change and how. The experiments compare open-weight and proprietary models under Static and Dynamic settings. Dynamic access improves Event discrimination for some models, but predicting the actual technical change remains difficult. The analysis also shows that finding related mechanisms in the literature does not necessarily help predict the mechanism that appears in the target period.

Critical strengths
  1. Besides reporting forecasting scores, this paper analyzes whether the predicted mechanisms appear in the target period. Dynamic forecasts match more mechanisms in the scientific record, but do not show a reliable increase in target-window matches. This separates finding plausible or related mechanisms from actually forecasting the future transition.
  2. The paper includes several analyses of where the forecasting signal comes from. The authors compare publication activity with graph relations and recency, and further test additional reading, re-answering, and evidence collected by stronger agents. The latter experiments show that providing more evidence does not reliably improve mechanism prediction.
Critical weaknesses
  1. The benchmark labels depend on automatically constructed method identities and evolution relations, but the construction audit shows disagreement on some accepted graph elements. In the GPT-5.5 audit, 43.3% of the audited identity pairs are judged as the same method, and 50.8% of the audited evolution edges retain the lineage or substitution label. Since these graph elements define the Event labels and Content references, the current human validation is relatively limited.
  2. The test windows extend from 2024 to 2026, while the knowledge cutoffs of several evaluated models are unknown. The paper includes a temporal analysis and explicitly notes that it cannot rule out contamination. This makes it difficult to determine whether the results reflect forecasting from historical evidence or prior exposure to later papers.
Questions for authors
  1. How do the construction audit results affect the reliability of the Event and Content evaluation?
  2. For models with unknown knowledge cutoffs, how do you distinguish forecasting from possible prior exposure to papers in the forecast window?
5 comments
AuthorsOpenReview ↗

Response to Reviewer 7ef4 (1/2)

Thank you for highlighting our distinction between proposing plausible mechanisms and forecasting realized transitions, and our analysis of which features help predict those transitions. Our responses are as follows:

Q1: How do the construction-audit results affect the reliability of the Event and Content evaluation?

A1: Thank you for raising this question. A link to the wrong source method can affect both its Event label and the reference used to score a Content forecast.

Reading of the construction audit. In the paper’s construction audit (Appendix C.6), GPT-5.5 re-examined sampled method pairs merged in the graph and recorded evolution edges. It judged 43.3% of the pairs to describe the same method and 50.8% of the edges to represent lineage or substitution. Both rates are weighted and include unresolved cases in the denominator. Among rejections, the most common disagreement concerned method specificity. Of the 179 audited edges, 72 qualified as targets for the Event task because the successor’s first paper documented its relation to the source within the window (Eq. 1). GPT-5.5 retained 51 of these, left 12 unresolved and rejected nine. Of the 33 edges rejected over method specificity, 30 fall outside this rule. These disagreements therefore rarely define evaluation targets, although they remain in the graph that forecasters can query.

To measure errors among the actual targets, we checked the evaluation targets against their papers through cross-model and human review. We then tested whether the main findings hold on the targets supported by each review.

  • Cross-model evaluation. We used the positives from the 600 matched Event pairs shared across models (common-600, Appendix D). Given the same evidence, Qwen3.8-27B (also the construction model), GPT-6.1-Sol and DeepSeek-V4-Flash-0731 checked the transition and the two Content fields against verbatim quotes. The fields are Where (the affected aspect of the source method) and What (the successor’s defining technical change). They supported 486, 367 and 241 targets, respectively. With forecasts and judge scores fixed, we repeated the main comparisons on targets supported by at least two verifiers, then on those supported by both GPT-6.1-Sol and DeepSeek, which excludes the construction model’s vote (Table 1). Event pairs were also dropped if a retrieved candidate for the negative qualified under the same rule. For Event, all four Dynamic AP gains remain positive, but only one 95% confidence interval excludes zero. Adding graph relations significantly improves AP on both subsets. For Content, the gap between Where and What scores remains significant for the same models as in the full set.

Table 1. Main findings on verifier-defined subsets.

FindingFull common-600≥2 of 3 verifiersGPT-6.1-Sol and DeepSeek
Content targets / Event pairs600 / 600378 / 205203 / 143
Where > What, models with 95% CI above zero, Static / Dynamic (§4.3)8/8 / 7/88/8 / 7/88/8 / 7/8
Mean Static What (§4.3)1.171.181.17
AP gain from adding graph relations to activity (§5.1)+0.093+0.082+0.097
Dynamic − Static AP, Qwen3.8-27B / Gemini (§4.2)+0.044 / +0.033+0.088 / +0.031+0.023 / +0.035
  • Expanded human review. Human annotators reviewed 72 stratified positive targets from common-600 against their papers. For Event, they checked the relation and both method identities. For Content, they also checked whether Where and What aligned with the paper (Table 2A). Some targets attached a genuine change to a broad task category when the paper named a more specific method. For the Content comparison, we required a genuine transition and at least partial support for the source method’s identity. We excluded a target if the review rated the successor’s identity, Where, or What as unsupported. Both Content findings hold on the 57 targets retained by human review (Table 2B).

Table 2A. Human review of 72 positive targets.

Audit checkResult
Genuine evolution71/72
Event: evolution and both identities supported (full or partial identity support)60/72 (83.3%)
Content: both Where and What aligned with the paper63/72 (87.5%)
Targets retained for Content evaluation57/72 (79%)
Agreement on evolution (20 independently reviewed by both annotators)20/20
Agreement on retention (same 20 targets)16/20 (κ = 0.57)

Table 2B. Content findings after human review (§4.3).

FindingFull common-600Targets retained after human review (57)
Where > What, models with 95% CI above zero (Static / Dynamic)8/8 / 7/88/8 / 7/8
Mean What score, Static1.171.15
AuthorsOpenReview ↗

Response to Reviewer 7ef4 (2/2)

A1 (continued). Sensitivity to label corrections. We also kept the forecasts fixed and changed the labels themselves for the two models with significant Dynamic gains in §4.2 (Table 3). We use pairs with valid forecasts in both modes (592 for Qwen3.8-27B, 533 for Gemini) and bootstrap over source methods for 95% CIs. After we corrected all 28 confirmed omissions, Dynamic still outperformed Static on Event AP for both models. When many more negatives change, as in the two stress tests, the Qwen3.8-27B gain stays at +0.020 or above, while the Gemini gain falls to +0.004–0.016. The Gemini gain is therefore less robust to label errors, and we will report both models on the repaired labels. Our response to Reviewer qkve, Q2 gives the corresponding §5.1 results for graph and publication-history features.

Table 3. Dynamic − Static Event AP under label corrections.

Event labels used for scoringQwen3.8-27BGemini
Original labels+0.044+0.033
Correct 23 human-confirmed omissions (full identity support)+0.048+0.031
Also correct five with partial identity support (28 total)+0.051 [+0.020, +0.078]+0.029 [+0.003, +0.056]
Treat all 261 machine-flagged negatives as positive (stress test)+0.026+0.004
Relabel 261 negatives drawn at random (mean of 200 draws)+0.020+0.016

For the effect of adding observed in-window successors to the Content references, please refer to our response to Reviewer CdkW, Q4.

We will add these audits to Appendix C, report verified-subset results alongside the originals and release per-task quality flags.

Q2: For models with unknown knowledge cutoffs, how do you distinguish forecasting from possible prior exposure to papers in the forecast window?

A2: Thank you for raising the question of prior exposure. We use the provider’s knowledge cutoff when available. For open models with an undisclosed cutoff, the weight release bounds possible pretraining exposure to public papers. The checkpoint may have seen papers available by then. Papers first made public later fall outside its training period.

We exclude the three-month window containing the boundary and take up to two complete quarters on each side, choosing those closest to it. Both GPT-5.5 settings share the December 1, 2025 cutoff. Qwen3-4B and Qwen3-8B were released in April 2025. The cutoff for Gemini 3.8 Flash and the weight release for Qwen3.5-9B both fall in March 2026, leaving one later quarter (2026Q2).

All forecast windows began after the December 2023 knowledge cutoff shared by Llama-3.1-8B and Llama-3.2-3B and ended before the releases of Qwen3.8-27B (August 2026) and DeepSeek-V4.1-Flash (September 2026). These two groups bracket the exposure question on the same targets. The Llama models could not have seen any forecast-window paper, while Qwen3.8-27B and DeepSeek may have seen all of them. Their mean Static What scores on common-600 were nearly identical (1.18 and 1.21 vs. 1.20 and 1.20, §4.3).

Table 4. Scores before → after each boundary.

ForecasterPeriods (before → after)AUROC (Static)AUROC (Dynamic)What (Static)What (Dynamic)
GPT-5.525Q2–Q3 → 26Q1–Q20.572 → 0.5350.612 → 0.5601.21 → 1.231.26 → 1.27
Codex + GPT-5.525Q2–Q3 → 26Q1–Q20.599 → 0.5590.625 → 0.5941.21 → 1.301.14 → 1.23
Qwen3-4B24Q4–25Q1 → 25Q3–Q40.513 → 0.4530.486 → 0.4961.20 → 1.181.29 → 1.25
Qwen3-8B24Q4–25Q1 → 25Q3–Q40.573 → 0.5480.518 → 0.4841.23 → 1.191.23 → 1.22
Gemini 3.8 Flash25Q3–Q4 → 26Q20.587 → 0.5450.603 → 0.6021.12 → 1.081.14 → 1.05
Qwen3.5-9B25Q3–Q4 → 26Q20.548 → 0.4950.498 → 0.5871.12 → 1.081.16 → 1.06

Event. On complete common-600 pairs, Static AUROC was lower in the later periods, while Dynamic changes went in both directions. The two periods contain different tasks, so a raw change mixes possible exposure with task difficulty. For GPT-5.5, Appendix L adjusts for this by subtracting the mean AUROC of Qwen3-4B and Qwen3-8B on the same valid pairs in each period. The 95% intervals for all four adjusted changes included zero (with and without Codex, in Static and Dynamic).

Content. Even in the periods before each boundary, when exposure is possible, mean What (missing answers scored as 1) stayed between 1.12 and 1.29 out of 5, and changes across the boundary ranged from −0.10 to +0.09. Possible exposure therefore did not help forecasters recover the realized technical change.

We will add the Event and Content comparisons to Appendix L and identify the models for which we use the weight release date as a proxy for the knowledge cutoff.

We would like to thank you again for your comments and suggestions, and would be open to further questions and discussions.

Dear Reviewer 7ef4,

Thank you sincerely for your time and effort. With ICLR receiving a record number of submissions this year, we know the workload on reviewers is especially heavy, and we truly appreciate your careful review.

As the reviewers currently hold differing views on our paper and the discussion period closes tomorrow (November 18), we would greatly value your further thoughts. In our November 13 response and revised PDF, we addressed each of your points --- specifically verifying our main findings across cross-model and expanded human-validated subsets (including label-correction sensitivity tests) and bounding prior exposure via pre-/post-cutoff comparisons using weight-release proxies and difficulty-adjusted baselines.

If any concerns remain, even a brief line would be hugely helpful, and we will gladly respond before the deadline.

Best regards,
The Authors

Comments on the paper

4 comments
AuthorsOpenReview ↗

General Response to All Reviewers

We thank all three reviewers for their careful reading and for recognizing the value of forecasting specific changes to scientific methods. In response to your concerns, we verified recorded transitions, tested how missed successors affect both tasks, and examined publication timing and possible prior exposure.

Verifying transitions and testing the main findings. In our expanded human review, the papers supported the transition and both method identities for 60 of 72 positive targets (83.3%), counting full or partial support for each identity. Three models also reviewed the targets against the papers. On both model-verified and human-reviewed subsets, forecasters still scored higher on Where (the limitation) than on What (the realized technical change), as in §4.3. On model-verified Event subsets, graph relations still improved prediction over publication activity alone (§5.1).

Checking for missed successors and their impact. Human review identified in-window successors for some Event negatives. After we corrected the confirmed omissions, the Dynamic gains reported in §4.2 remained positive. On the full Event set, the average precision gain from graph relations changed from +0.064 to +0.062 (§5.1). To improve negative selection, we replaced flagged negatives in the shared evaluation subset with matched alternatives screened for successors.

For Content, we added references for other model-verified successors in the same window. Rescoring the same forecasts on those tasks raised mean What from 1.20 to 1.55. Most gains reflected partial matches. Even with expanded references, only 1.7% of outputs scored 4 or 5 for predicting the technical change (§4.3).

Assessing timing and prior exposure. For all 600 positive targets audited, the earliest public record we identified fell within the forecast window. We found potential post-cutoff information or a paper mismatch in 3.5% of the Static abstract occurrences we could check. After excluding affected targets, Where still scored higher than What. Mean What also remained low on both sides of model cutoffs or weight releases.

We will report these validation results and their implications in the revised manuscript. We will apply the successor screening to every Event negative, release the repaired labels as the official version and report the main tables on them, keeping the original labels in the appendix. We will also share the expanded Content references with supporting papers.

AuthorsOpenReview ↗

Summary of the revised PDF

We thank the reviewers for their careful reading and constructive suggestions. We have uploaded a revised PDF with changes marked in blue. The revision covers two aspects:

  1. Additional validation. We verified the evaluation targets with three models and two human annotators and tested the main findings on the verified targets (Appendix C.6.1, Reviewers 7ef4, qkve and CdkW). We screened and human-reviewed Event negatives for missed successors, measured the effect of label corrections, and repaired the common-subset negatives (Appendix C.8, Reviewers qkve and CdkW). We also scored Content forecasts against additional observed successors (Appendix F.3, Reviewers CdkW and qkve) and audited abstract revisions and knowledge-cutoff boundaries (Appendices C.1 and L, Reviewers 7ef4, qkve and CdkW).
  2. Improved clarification. We clarified that transitions record author-reported changes and that Event labels date first public disclosure (§3, Reviewer CdkW), stated the question each analysis addresses (§5, Reviewer CdkW), and added the body-text re-extraction, a summary of all human review, and the new prompts (Appendices C.7, F.4 and O.10, Reviewers CdkW, qkve and 7ef4).

The main tables still use the original labels. As stated in our responses, we will apply the screening to every Event negative and report the main tables on the repaired labels in the final version.

Area_Chair_NegSOpenReview ↗

Reminder

Dear reviewers,

Please review the authors’ responses carefully and discuss with the authors if you have more concerns or questions. If their responses have changed your assessment, please consider revising your scores accordingly.

AuthorsOpenReview ↗

Summary of the Discussion

We thank the reviewers and the Area Chair for their time. Reviewer 7ef4 confirmed that the expanded human review and the verified-target results address the concern about the benchmark labels, Reviewer CdkW indicated that the main concerns have been largely addressed, and Reviewers CdkW and qkve updated their evaluations. We briefly summarize how our responses and the revised PDF address the main concerns.

  1. Reliability of the evaluation targets (Reviewers 7ef4, qkve and CdkW). Three models and two human annotators verified the targets. The papers support the transition and both method identities for 60 of 72 reviewed targets. On the verified targets, models still identify the affected aspect of a method (Where) more reliably than the realized technical change (What), and graph relations still improve Event prediction beyond publication activity (Appendix C.6.1).
  2. Missed successors and Event negatives (Reviewers qkve and CdkW). We estimated how often negatives miss a successor, showed that the gains from Dynamic access and from graph relations stay positive after correcting confirmed omissions, and repaired the common-subset negatives (Appendix C.8). We will apply this repair to every Event negative and report the main tables on the repaired labels.
  3. Single Content reference (Reviewers CdkW and qkve). We added 721 model-verified references from other successors observed in the same windows, 16 of which were confirmed by human review, and rescored the original forecasts with the judge unchanged. Mean What rose from 1.20 to 1.55, mostly through partial matches, while only 1.7% of outputs identified the defining technical operation (Appendix F.3). Low What scores therefore reflect the difficulty of anticipating the specific change, not only the use of a single reference. We will release these references with their supporting papers.
  4. Timing and prior exposure (Reviewers 7ef4, qkve and CdkW). Each successor is dated by its earliest public record, so the label refers to first public disclosure. Substantive later revisions affect 3.5% of the checked abstracts in model inputs, and excluding them leaves the main findings unchanged (Appendix C.1). What scores stay low even before each model’s cutoff, when exposure is possible, and models that may have seen every forecast-window paper score no higher than models that could not have seen any (Appendix L). As Reviewer 7ef4 noted, these checks bound but do not rule out an effect of prior exposure, and we will state this limitation in the final version.

We thank the reviewers again for feedback that has substantially improved the paper.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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