- Rating
- 3(+1)
- Confidence
- 4
- Informativeness
- 2
- Presentation
- 3(+1)
- Soundness
- 2
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Paper summary
The paper presents BCG-FM, a contrastive foundation model for bed-based BCG. It is pretrained on about 2.04M hours of night recordings of a commercial sleep sensor, using the participant-level InfoNCE framework. The model is evaluated on the biological age estimation task, self-reported condition classification task, and externally on two small public BCG datasets
Critical strengths
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The topic is highly relevant in the field of Biosignal Foundation models. Bed-based BCG is under-explored in the foundation-model literature, and the dataset is far larger than any previous BCG study. The work filled the gap by creating a foundation model for the BCG signal.
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The data come from a commercially deployed consumer sensor that needs no user action after setup. This makes long-term, low-burden monitoring realistic, including for groups who struggle to wear devices, such as older adults.
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Figure 1 summarises the whole pipeline in one place with good quality: sensor and channel decomposition, positive-pair construction, the student–teacher architecture, embedding aggregation, and the downstream tasks, alongside the main results.
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Potential resource contribution. The authors promised to release the Twilight dataset with fixed splits and evaluation scripts. Paired BCG–PSG data of this kind is very rare and valuable for the development of this field.
Critical weaknesses
- The paper claims to be " the first foundation model for ambient mechanical biosignals”, but writs PPG and accelerometry are also recorded passively and continuously once the device is on. The bed sensor itself also needs initial setup. So “ambient vs. wearable” is more of a difference in form factor, not in user effort. IMU foundation models are therefore direct prior work on mechanical biosignals. For example, here are some related works the author can consider referring to:
Yuan, H., Chan, S., Creagh, A.P., Tong, C., Acquah, A., Clifton, D.A. and Doherty, A., 2024. Self-supervised learning for human activity recognition using 700,000 person-days of wearable data. NPJ digital medicine, 7(1), p.91.
Erturk, E., Kamran, F., Abbaspourazad, S., Jewell, S., Sharma, H., Li, Y., Williamson, S., Foti, N.J. and Futoma, J., 2025. Beyond sensor data: Foundation models of behavioral data from wearables improve health predictions. ICML 2025.
Gu, X., Shu, Y., Han, J., Liu, Y., Liu, Z., Anibal, J., Sangha, V., Phillips, E., Segal, B., Yuan, H. and Liu, F., 2025. Foundation models for biosignals: A survey.
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In the contribution part, the authors used the result: atrial fibrillation (0.954) to suggest the model can accurately estimate disease. However, in Table 5, demographics alone reach an AUROC of 0.994 for AF classification (which I find very strange), 0.040 higher than BCG-FM.
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Some information in Table 1 seems inconsistent and needs clarification. Disease (Train) have fewer participants than Pretrain (50,128 vs. 136,575) but more segments (168M vs. 122M) and more hours (2,793,434 vs. 2,041,288), despite Disease being described as a “pretrain subset”. The total hours of Disease Train + Disease Test (3.49M) even exceeds the total hour listed in the bottom row (2.75M). It is very unclear to me how these numbers in Table 1 add up. Also, the signal-quality filtering rules are not described for the pretraining cohort. Why is signal quality filtering only needed for pretraining but not for finetunning? External Dataset 1 has 153 sessions, 153 segments and 2.5 hours, which means each segment is only about 1 minute. Section 3.1 described External Dataset 1 as 153 nights, which does not appear to be "overnight", so it does not test the paper's central claim. Please add a column to Table 1 reporting the mean or median recording length per session and std, and state whether a session is one night.
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“The first to show that BCG supports general-purpose health prediction” is a bit overstated. BCG has a substantial prior literature on heart rate, sleep, and heart-failure monitoring. For example:
Sadek, I., Biswas, J. and Abdulrazak, B., 2019. Ballistocardiogram signal processing: a review. Health information science and systems, 7(1), p.10.
Aydemir, V.B., Nagesh, S., Shandhi, M.M.H., Fan, J., Klein, L., Etemadi, M., Heller, J.A., Inan, O.T. and Rehg, J.M., 2019. Classification of decompensated heart failure from clinical and home ballistocardiography. IEEE Transactions on Biomedical Engineering, 67(5), pp.1303-1313.
In addition, the two external datasets used in this study were themselves released for BCG-based cardiac assessment.
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Baseline models trained with traditional domain features such as overnight heart rate, HRV, respiratory rate, etc are missing as a comparison.
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In the Discussion section, the authors attributed the performance improvement to four times more pretraining hours and participant-level pretraining across nights compared to other models, but there are no results to support this claim. Each row of Table 3 uses a different dataset, population, age range, and health definition, so the MAEs are not directly comparable.
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The experiment results have no standard deviations or confidence intervals. It is unclear if the improvements are significant or not. Please report seeds or bootstrap 95% CIs and paired tests, plus prevalence and number of positives per task.
Questions for authors
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The paper described that the supervised E2E baseline was trained with 3372 users, why can't it be trained with all 136K users, the same as the BCG-FM?
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The paper compared the BCG-FM biological age prediction performance to the PpgAge, ECG-age, and Brain-age papers, but only showed its accuracy in age estimation. However, the value of biological age is more about the age gap (predicted biological age - chronological age) and its association with health outcomes rather than the accuracy of age estimation. Could the author report MAE and the bias-corrected age gap in the non-healthy tiers and the disease cohort, and test the association of the gap with the different conditions?
4 comments
Thank you for the detailed reply and the additional results. Most of my concerns have been addressed. Two points remain:
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In Table A, all hand-crafted baselines score below demographics alone. The more informative comparison is therefore against demographics plus domain features. Could the authors report the AUROC for demographics + hand-crafted signal features, ideally with paired confidence intervals? This would show how much BCG-FM adds beyond what demographics and standard physiological features already provide. It would also support the statement that adding the features to BCG-FM does not add information.
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The authors explain that AF in External Dataset 1 is confounded by age: there are 4 AF subjects aged 71–91 in a cohort with median age 48, and age alone gives AUROC 0.975. This dataset therefore cannot support an AF-detection claim, as the authors note. The embeddings-only AUROC of 0.941 is also likely driven by the age information the embeddings carry. Would the authors remove AF detection on External Dataset 1 from the contributions, abstract and conclusion?
Thank you for the follow-up and acknowledgement of resolved concerns.
- In Table B we compare BCG-FM to signal and device baselines with and without demographics. All arms use the same split, probe and 64 sampled minutes per user. Demographics are age, sex and BMI.
Table B
| Arm | Macro AUROC [95% CI] | Paired Δ vs BCG-FM [95% CI] |
|---|---|---|
| BCG-FM + demographics | 0.696 [0.687, 0.704] | reference (+ demographics) |
| BCG-FM (embeddings only) | 0.686 [0.677, 0.694] | reference (no demographics) |
| Signal features + demographics | 0.674 [0.665, 0.683] | −0.022 [−0.029, −0.015]* |
| Device outputs + demographics | 0.671 [0.662, 0.680] | −0.025 [−0.032, −0.017]* |
| Demographics | 0.658 [0.650, 0.667] | −0.037 [−0.046, −0.029]* |
| Signal features | 0.605 [0.596, 0.615] | −0.081 [−0.090, −0.071]* |
| Device outputs | 0.577 [0.567, 0.587] | −0.109 [−0.119, −0.099]* |
Macro AUROC over 14 conditions; Δ = arm − BCG-FM with the same demographics setting; paired 1,000-rep user bootstrap; * 95% CI excludes 0.
Adding the signal features to BCG-FM + demographics changes macro AUROC by −0.001 [−0.002, 0.000].
- AF on External Dataset 1. We agree. We will remove AF detection on External Dataset 1 as a claim and any mention in the abstract, contributions and conclusion.
We hope these additions address your remaining concerns and that you will consider adjusting your score accordingly.
Thank you for your detailed response. I appreciate the additional results. I will raise my score to 3.
Thank you for the constructive review. The new baselines are in Table A under CW5.
CW1.
We have dropped both "first" claims. We would keep one narrow distinction for "ambient": after a one-time setup, a bed sensor records every night with nothing to wear or charge, whereas a wrist device records only while it is worn and charged. We agree this is a difference in form factor and now present it that way. IMU models use a different sensor (a wrist accelerometer rather than a piezoelectric sensor under the body) but capture related mechanical information, so §2 now discusses them as prior work (Yuan et al., 2024; Erturk et al., 2025; Gu et al., 2025).
§2 also covers Sadek et al. (2019) and Aydemir et al. (2019) as prior BCG work, and states that both external datasets were released for BCG-based cardiac assessment.
CW2.
The 0.994 is an age effect. External 1 has only 4 AF subjects, aged 71, 74, 75 and 91 in a cohort with median age 48, so age alone gives 0.975. This cohort cannot validate AF detection, though embeddings alone reach an AUROC of 0.941 (0.954 with demographics).
CW3.
In Table 1 the Disease and Healthy rows count every in-bed and out-of-bed minute of a session, while Pretrain counts only quality-filtered in-bed minutes; "pretrain subset" refers to subset of the pretrain participants that has self-reported disease labels. The Total row adds Pretrain, Healthy and External only. We filter in pretraining to keep contrastive pairs clean and embed all minutes downstream, as in deployment; the filter rules are now in the appendix. Table 1 now has a minutes-per-session column (mean ± SD): Pretrain (sessions with data) 477 ± 163, Healthy (Train) 777 ± 270, Disease (Train) 620 ± 190, Twilight 475 ± 47 in bed, External 2 629 ± 89.
External 1 consists of 153 short recordings (20–45 s, 1–3 per subject) rather than nights; Table 1's 2.5 h counted each as a padded 60-s input. §3.2 is corrected and we now present it as a short-segment transfer test.
CW4.
See CW1.
CW5.
We added hand-crafted baselines under the same probes and splits: 21 signal features (band powers, HR, RR, HRV, movement) and the device's own HR/RR/HRV/sleep outputs.
Table A (BCG-FM age = Table 2 Ridge row)
BCG-FM is ahead of all baselines across 14 conditions (irregular heartbeat, with one test positive, is dropped), and adding the features to BCG-FM is not adding information. General and cardiac foundation models (Chronos, MOMENT, PaPaGei) are 2.2–2.7 years behind on age.
CW6.
Both attributions are removed and Table 3 is presented as context. We did not ablate cross-night positives, so we make no claim about them. For data scale we ran a controlled ablation with batch size 384: with 1%, 10% and 100% of the pretraining devices, validation age R² is 0.404 / 0.436 / 0.458 and Twilight staging κ 0.269 / 0.357 / 0.415.
CW7.
Tables now give n, n+, prevalence and 95% subject-bootstrap CIs, with paired tests against baselines. Examples: age MAE (Transformer head, ages 18–70) 3.26 [3.17, 3.34] yr; External 2 AF per window 0.699 [0.578, 0.811]; External 1 heart failure (embeddings only) 0.841 [0.72, 0.94] with 7 positives. Pretraining is a single run per configuration, so the intervals cover test-set sampling only.
Q1.
By design the age model is trained only on the healthy cohort, so that predicted age reflects healthy ageing. A supervised model trained on all 136K users would learn a different target, age in a population that includes disease. Pretraining needs no labels, so it can use everyone. With 500 labelled users the frozen probe (4.38 yr) already outperforms the supervised model trained on 3,372 (4.41 yr).
Q2.
We tested the bias-corrected age gap on 63,065 participants outside the healthy cohort, adjusting for age and sex. A larger gap is associated with 8 of 14 conditions (FDR < 0.05): OR per SD is 1.14 [1.12, 1.17] for hypertension, 1.09 for heart conditions and for snoring, and 1.08 for asthma/COPD. Diabetes, thyroid disorder and cancer show no association.
The gap also grows with the number of reported conditions: +0.21, +0.49, +0.59 and +0.93 yr for 0, 1, 2 and 3+ (+0.29 yr per condition [0.25, 0.33]). MAE (ridge probe) is 4.19–4.45 yr across these groups against 3.80 on the healthy test set (Table 2), and 4.32 yr with a mean gap of +0.66 yr in the disease cohort (≥ 1 condition). Effects are modest and labels self-reported, so we read this as supportive evidence only.