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Withdrawn from ICLR 2027

Cross-Trajectory Semantic Credit Sharing for Mathematical Reasoning

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Outcome-supervised methods such as GRPO assign one advantage throughout each response, even when solutions with different final outcomes contain the same local mathematical derivation. Prefix-based branching pools terminal feedback through shared generation histories, yet related local derivations can also arise in independently generated solutions. We introduce Semantic Credit Sharing (SCS), which forms local sharing groups after rollout collection. To match related content expressed in different forms, a frozen encoder represents selected segments using their original text, preceding context, and auxiliary normalized mathematical expressions. SCS clusters these segments within each question, averages the advantages of the distinct responses represented in each cluster, and applies the resulting coefficients to the matched token spans. Other token advantages remain unchanged. Sharing reuses the terminal rewards of the sampled responses. Across three independent training runs on Qwen3-1.7B-Base, SCS improves mean accuracy across five benchmarks by 1.88 percentage points over Dr.GRPO. It also outperforms a within-response assignment-shuffling control by 1.10 points, demonstrating the value of preserving credit-to-segment correspondence. On Qwen3-4B-Base, a single paired run yields a 1.49-percentage-point improvement over Dr.GRPO. These results show that local mathematical content can support feedback sharing beyond common generation histories.

Primary area:
reinforcement learning
Keywords:
reinforcement learning, mathematical reasoning, credit assignment, RLVR

Reviews

Among:
Shape:
1234this paper, Bottom 10%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_QdhGOpenReview ↗
Rating
2
Confidence
4
Informativeness
2
Presentation
3
Soundness
1
Read review
Paper summary

SCS shares outcome-based advantages among corresponding mathematical segments in independently sampled solutions. A frozen encoder identifies related segments, and rewards from their source responses are pooled to update the matched token spans. The method improves average accuracy over Dr.GRPO across three 1.7B runs and in an additional 4B comparison. A within-response shuffling control supports the usefulness of applying shared credit to its original matched locations.

Critical strengths
  • S1. Reusing completed solutions to improve local feedback is an appealing idea. The method preserves independent sampling and does not require extra continuations or process-level labels.

  • S2. Three training runs, consistent paired improvements, and the assignment-shuffling control provide credible evidence that the method helps in the tested setting.

  • S3. The paper reports costs, imperfect matches, and the limited fraction of tokens whose advantages change. This makes the contribution easier to assess and avoids presenting approximate semantic matching as exact equivalence.

Critical weaknesses
  • W1. The contribution of SCS's mathematical-correspondence mechanism is not sufficiently isolated from post-rollout advantage sharing itself. The Dr.GRPO comparison shows the benefit of introducing local advantage sharing, and SCS-shuffle provides evidence that pooled credit is more effective when applied to its semantically matched locations. However, neither comparison isolates what the proposed correspondence construction—particularly the use of preceding context and normalized mathematical representations—adds over a simpler segment-matching scheme. This distinction is important because the paper explicitly builds on prior post-rollout advantage sharing, while the main methodological novelty lies in how local mathematical correspondence is established. A controlled ablation that keeps candidate selection, clustering, and the advantage-sharing rule fixed but simplifies the matching representation, for example by using only the current raw segment without preceding context or normalized mathematical fields, would more directly establish the contribution of the proposed correspondence design.

The relationship to prior cross-trajectory grouping methods could also be clarified. In particular, GiGPO (NeurIPS 2025, Sections 4.2–4.3) similarly constructs local groups from completed trajectories without requiring additional rollouts, but is not discussed in Related Work or Table 3. GiGPO groups repeated environment states and compares action returns within those states, whereas SCS groups approximately corresponding mathematical segments and shares coefficients using terminal outcomes relative to a question-level reference. These are substantive differences, so GiGPO is not necessarily a directly interchangeable baseline; nevertheless, explicitly positioning SCS relative to this line of work would make the novelty boundary clearer.

  • W2. The semantic correspondence at the core of SCS lacks direct validation of whether grouped segments are sufficiently compatible to share credit. Downstream gains, the assignment-shuffling control, and outcome-prediction diagnostics provide useful evidence, but do not measure matching precision or the prevalence of mathematically incompatible pairs. Figure 4(b) makes the concern concrete: a valid rearrangement and a wrong-sign equation enter the same cluster, weakening the negative coefficient on the erroneous equation. The paper openly acknowledges such mismatches and correctly limits the interpretation of its leave-one-out diagnostic; nevertheless, the frequency and training relevance of these errors remain unknown. Because grouping changes policy-gradient coefficients, a small contextual matching-quality evaluation is needed to assess the reliability of the mechanism, rather than relying only on aggregate performance and terminal-outcome predictiveness.
Questions for authors
  • Q1. Could the authors include GiGPO in Related Work and Table 3 and explain the differences in grouping units, local reference, and advantage construction? An empirical GiGPO-style comparison would be useful only if states and actions can be defined fairly in this mathematical setting; otherwise, a clear methodological comparison would suffice to establish the boundary. Q2 asks for a directly applicable control of the correspondence design.

  • Q2. How much of the improvement remains if the frozen encoder receives only the current raw segment, without the preceding context or normalized mathematical fields, while keeping candidate selection, clustering, and the advantage-sharing rule unchanged?

  • Q3. Could the authors evaluate matching quality on a representative sample of accepted pairs, with the preceding context available to annotators? Distinguishing compatible derivations from surface similarity and incompatible equations, and reporting how often mismatches actually change advantages, would directly complement the outcome-prediction diagnostic. Exact textual identity or universal mathematical equivalence need not be the criterion.

  • Q4. How sensitive is SCS to KK, τ\tau, and λ\lambda? In particular, beyond limiting replacement to matched spans, what supports fixing λ=1\lambda = 1 rather than retaining some response-level credit? A small sensitivity study could show how these choices affect matching coverage, precision, and downstream performance, especially in the presence of the recorded mismatches.

  • Q5. Which kinds of mathematical problems or recurring derivations benefit most from sharing? Given that only a small fraction of tokens receive changed advantages, representative successful cases could help explain where those local changes produce the observed gains.

Reviewer_fQVEOpenReview ↗
Rating
1
Confidence
4
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

In this paper, the authors propose Semantic Credit Sharing (SCS), a method that shares advantages across independently sampled responses in GRPO-style RLVR for math reasoning. The motivation is that two responses can contain the same intermediate step (e.g., both derive ab = 6) but end with different final answers, so under GRPO the same step gets opposite advantages.

After rollout, SCS splits each response into segments and picks up to 4 candidates per response. It embeds each candidate with a frozen Qwen3-Embedding-0.6B, together with the previous segment and some normalized math expressions, and runs complete-link clustering within each question (threshold 0.90). For each cluster that covers at least two responses, the authors average the rewards of those responses and use q_C − p_x as the new advantage on the matched tokens. Since λ = 1, this fully replaces the original advantage on those tokens. Other tokens are unchanged, and no extra rollouts are needed.

The main experiments train Qwen3-1.7B-Base for 400 steps with 3 runs per method. SCS gets a five-benchmark average of 51.92. That is 1.88 points above Dr.GRPO, 1.10 above SCS-shuffle (a control that swaps cluster assignments within the same response), and 0.56 above DAPO w/o DS. On Qwen3-4B-Base there is only one run, where SCS is 1.49 points above Dr.GRPO. All test numbers come from one greedy decode per question. The appendix also reports how many tokens are actually changed (around 2%), the extra cost (+12.9% GPU-hours), and an analysis showing that cluster peers predict a response’s reward better than the same number of random peers.

Critical strengths
  1. The shuffle control is well designed. It keeps the same clusters, the same pooled rewards and almost the same number of changed tokens (1.95% vs. 2.03%), and only changes which spans receive the shared credit. SCS is better than SCS-shuffle in all three paired runs (+1.21, +1.20, +0.88). This is the main evidence that where the credit goes matters, and it is the main reason I am not giving a clear reject. The reporting is also very transparent: per-run results, selected checkpoints and dev-set counts are all in the appendix.
  2. The idea is simple and practical. It shares credit based on what a step says instead of on a shared prefix, so it needs no tree rollouts or extra sampling. It can be added to an existing GRPO pipeline with moderate overhead.
Critical weaknesses
  1. The experiments do not show that the semantic matching itself is what helps. SCS-shuffle keeps the same source responses for every cluster, so it can only test where the credit is placed. It cannot test whether grouping by semantic similarity is better than grouping at random. Also, SCS-shuffle alone already gets +0.79 over Dr.GRPO, so part of the gain may simply come from pulling advantages toward the group mean on about 2% of tokens. I would like to see (a) random clusters across responses with the same cluster sizes and coverage, and (b) the same amount of advantage shrinkage applied to random spans.

On top of that, there are no ablations for λ, τ, K, the encoder, the normalizer or the context field. There is also no measurement of how often the clusters are actually correct, and Figure 4(b) already shows a sign-error equation grouped with a correct one. Finally, Appendix F shows that the mean over all 15 other responses predicts the reward better than the cluster peers. This makes me unsure why λ = 1, which fully replaces a response’s own reward, is the right choice.

  1. The evaluation is too noisy for the size of the gains. Each test number comes from a single greedy decode per question (Section 3, Table 9), so it is basically accuracy with n = 1. RLVR math papers usually sample at least 8 (often 16 or 32) responses per question and report the average pass@1. With only one decode, we cannot tell whether a 1–2 point difference is a real improvement or just luck. This is especially true on AMC83, where one question is worth 1.2 points. Also, the “n = 3” in Table 1 means three training runs, not three evaluation samples, so each standard deviation comes from only three numbers. The 4B result is a single run.

I am also not sure the current models and benchmarks can show much even with better evaluation. Both policies are small Qwen3 base models (1.7B and 4B). Two of the five benchmarks (GSM8K and MATH500) are already close to saturated at this scale: even in this paper, the 4B model gets about 93% on GSM8K and 80–82% on MATH500, so there is little room left to see a difference between methods. Harder benchmarks are far from saturated. In other RLVR work, Qwen3-4B-Base trained with plain GRPO is still only around 15–20% on AIME24/25, so this is where a credit-assignment method should show its value. For reference, fully post-trained models of similar size are much stronger on AIME (e.g., Qwen3-4B-Thinking-2507 reports 81.3 on AIME25). I do not expect a 400-step run from a base model to match these models. My point is that a 1–2 point gain on near-saturated or very small benchmarks at 1.7B/4B scale says little about whether the method matters in practice. It would be more convincing to train at least one 7B/8B model, ideally also one from another model family, and to show clear gains on harder benchmarks such as AIME24/25.

The gains themselves are small and come mostly from AMC83. Without AMC83, the gain over Dr.GRPO drops from 1.88 to 0.75 (Table 5). The gain over DAPO w/o DS is only 0.56, and one of the three runs favors DAPO. Finally, SCS costs 12.9% more GPU-hours, but there is no compute-matched baseline. There is also no comparison with SALT (Li et al., 2026), which already averages advantages across trajectories after rollout.

Questions for authors
  1. Can you re-evaluate all methods with at least 8 samples per question (e.g., 16 samples at temperature 0.6–1.0) and report the average pass@1? Please do this for both the selected checkpoint and the last checkpoint (step 400). Can you also add harder benchmarks such as AIME24/25 and at least one larger model (7B/8B)? Since AIME has only 30 questions per year (one question is about 3.3 points), please use more samples there (e.g., 32 or 64). Does SCS still beat SCS-shuffle, Dr.GRPO and DAPO w/o DS in that setting? This is the result that matters most for my score.
  2. How does SCS compare with (a) random clusters across responses with the same sizes and coverage, and (b) the same amount of advantage shrinkage applied to random spans?
  3. What happens with λ = 0.5, with τ = 0.85 or 0.95, or without the normalizer or the previous-segment context?
  4. How does SCS compare with Dr.GRPO trained for the same GPU-hours, and with a SALT-style matching baseline?

Clarifications:

  1. If you manually check a sample of clusters, what fraction actually contain equivalent steps? For the roughly 0.95% of tokens whose advantage flips sign, how many come from wrong matches, and how many are correct steps that get a negative advantage because most responses containing them failed?
  2. In Appendix F, the mean over all 15 responses predicts better than the cluster peers. Given that, why use λ = 1 instead of a weight that depends on cluster size?
Reviewer_AWXLOpenReview ↗
Rating
2
Confidence
4
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

The paper introduces Semantic Credit Sharing (SCS), which redistributes outcome-based advantages among corresponding mathematical segments across independently sampled responses. A frozen embedding model represents selected segments using their original text, preceding context, and supported normalized mathematical expressions. Complete-link clustering forms correspondence groups within each question. Each group receives the average advantage of its distinct source responses, with each response contributing once regardless of repeated segments. The shared coefficient replaces the advantages at matched token spans, while unmatched tokens retain their original response-level advantages.

Critical strengths
  1. A practical mechanism for extracting local feedback from existing independent rollouts. SCS uses recurring mathematical content to organize feedback sharing after generation, allowing segments from different reasoning histories to benefit from pooled terminal outcomes. It requires neither additional prefix-conditioned continuations nor separately supervised process rewards.
  2. Controlled, repeated experiments support the importance of semantic credit placement.
Critical weaknesses
  1. The evaluation benchmarks appear relatively easy. Including competition-level benchmarks such as AIME would strengthen the evaluation.
  2. Only a small proportion of tokens appear to have their advantages modified through credit sharing, potentially limiting the method’s impact.
  3. Embedding similarity does not guarantee mathematical compatibility between expressions.
Questions for authors

The performance gains appear modest, particularly given the additional computational overhead. Do these gains justify the increased computational cost?

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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