acceptodds
Under review as a conference paper at ICLR 2027

Token Credit Assignment as a Boundary-Value Problem in RLVR

Abstract

Reinforcement learning with verifiable rewards (RLVR) provides sparse outcome-level feedback, while methods such as GRPO assign the same credit to every token in a response. With binary terminal rewards, exact local hindsight evidence and the initial value determine a Bellman value path whose increments are token advantages and whose endpoints fix their total budget. Motivated by on-policy distillation (OPD), teacher–student likelihood ratios provide surrogate evidence, but their bias and noise can cause the reconstructed path to violate this budget or value boundary. To reconstruct the Bellman value path guided by OPD, we propose three design requirements targeting the objective of RLVR, utilizing the information of OPD. These requirements lead to Endpoint-Locked Value-path Evidence Reconciliation (ELVER). ELVER-Affine projects raw credits onto the budget hyperplane in closed form, while ELVER-Box reconstructs a path with constrained value bounds, and it minimizes squared Euclidean distances to the evidence-induced transition lines, yielding a strictly convex quadratic program. Experiments on five mathematical reasoning benchmarks show that ELVER-Box outperforms standard methods.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Token Credit Assignment, Reinforcement Learning with Verifiable Rewairds, Language Model

Reviews

Among:
Shape:
1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_LbgdOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
3
Soundness
1
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Paper summary

The paper combines verifiable reward in RLVR and teacher guidance in OPD, and proposes ELVER, a token-level credit assignment method that reassigns the token advantage based on teacher likelihood. ELVER ensures three properties:

  • Endpoint consistency. The sum of token advantage equals the sequence advantage.
  • Uniform credit under neutral evidence. If the teacher likelihood suggests neutral evidence (local hindsight evidence near 1), the assignment should be close to uniform credit.
  • Probability bounds. The token value function should lie within [0,1] for binary reward setup.

The paper compares two variants of ELVER with Raw Value Recursion, GRPO and OPD on math benchmarks, covering both on-policy distillation and self-distillation scenarios. ELVER-Box outperforms all baselines on all the math benchmarks.

Critical strengths

None.

Critical weaknesses
  1. Missing baselines in experiments. The raw value recursion is an intermediate method proposed in the paper. GRPO is an RLVR approach without teacher guidance, OPD does not require verifiable reward signal. The paper does not compare with any published on-policy distillation method with verifiable reward, e.g., the paper mentioned in related work (Line 89-98). Specifically, OPDVR is closely related with the paper's approach and should be compared in experiments.
  2. The theoretical motivation does not support the method. According to my understanding, the paper's motivation is to estimate the advantage function (Proposition 1), and the teacher policy is used to estimate the hindsight probability. While this is an implicit assumption, the approximation is acceptable. However, this has no clear relation with the three design requirements (Line 210-215) that directly motivates ELVER. While the goals can be viewed as necessary for a valid advantage function, they are not sufficient. By constructing A^t\hat A_t as in ELVER-Affine or ELVER-Box, we are no longer approximating the real advantage function in RL, but constructing a sequence that looks like a reasonable advantage.
Questions for authors
  1. Can the authors justify why they fail to compare ELVER with OPDVR, RLSD and CSCR in experiments, given that they are acknowledged already as prior work?
  2. Does it make sense to treat ELVER as a pure heuristic credit assignment approach? I believe the method itself is reasonable, but I cannot agree to motivate it as an approximation to the real advantage function.
4 comments
AuthorsOpenReview ↗

Respone to Lbgd 1/2

Thank you for highlighting the need for a comparison of baselines with various seeds, and for asking us to clarify the relationship between our reconstruction criteria and the RL advantage. We have added an OPDVR comparison and two RL experiments with exact advantage references to the revised PDF.

Weakness 1. Missing baselines in experiments.

We have added OPDVR in the DeepSeek-R1-Distill-Qwen-1.5B setting. And to identify the contribution of Probability Bound we have added the Box-unbounded method, who keep the same with ELVER-Box but removing the box condition. The OPDVR and Box-unbounded experiment has been incorporated into Section 5 and Table 2 of the revised manuscript.

The experiment results show that

  • Simple combination of teacher signals and terminal signal may have little help for training for the thinking model. It may because lack of theoretical guarantee.
  • The minimizing objective of Box method is useful for training, as we could see the improvement of Box-unbounded compared to other method. Moreover, Goal III in our design or probability bound actually could improve the training performance which may correct the teacher bias.

We additionally train with three seeds under the DeepSeek-R1-Distill-Qwen-1.5B setting. All results use the same hyperparameters in the Appendix B.

MethodAMC 2023AIME 2024AIME 2025AIME 2026HMMT Feb. 2026Avg.
OPDVR66.25 ± 0.7122.29 ± 0.4424.90 ± 0.0023.49 ± 1.7013.97 ± 0.4730.18 ± 0.48
Box-unbounded75.06 ± 0.1933.23 ± 1.0332.92 ± 0.5933.44 ± 1.0319.22 ± 0.5438.77 ± 0.68
ELVER-Box80.60 ± 0.2836.70 ± 0.8434.37 ± 0.8935.31 ± 0.9619.29 ± 0.7141.26 ± 0.49

Weakness 2. How the three goals relate to approximating the exact advantage

We agree that our writing may get confused when reconstructing advantage functions. In our method, the theory of Hindsight Credit Assignment is the key to reconstruct the exact advantage functions (equation 8). Our main focus is on how to properly use the biased teacher evidence. So we propose three goals:

  1. Endpoint consistency enforces the telescoping identity of the true advantage, ∑tAtπ=R−V1π\sum_t A_t^\pi=R-V_1^\pi. This supplies a global constraint which guarantee the reward signal can be used.

  2. Uniform credit under neutral evidence specifies what the estimator does when the teacher supplies no local discrimination. This may explain the question if we do not have any prior intermediate information, what are the advantage like. Motivated by the success of group relative method and minimum energy intuition, we think that the uniform credit is the convergence when teacher evidence disappears.

  3. Probability bounds use the fact that Vtπ=Pr⁡π(R=1∣st)∈[0,1]V_t^\pi=\Pr_\pi(R=1\mid s_t)\in[0,1] under binary rewards. The bounds may provide the legal values during reconstruction. Our following experiments show the key role of it in reconstruction.

In general, to approximate the exact advantage is theoretically guaranteed by the HCA. The three goals are the proposed standard of designing an algorithm to properly use the biased teacher evidence.

Moreover for Box, Theorem 3 relates the reconstructed credits directly to Aπ\mathbf A^\pi. At the Box optimum, its bound reduces to

\le \sqrt{1+\frac{4b_1^2}{\lambda*}}|\widehat V_1^\pi-V_1^\pi| + \frac{2}{\sqrt{\lambda*}} ||\bar e(\mathbf V^\pi)||_2,$$ under the theorem's assumptions. It is that if we have good estimator of initial value and intermediate value, we can get the exact advantages.
AuthorsOpenReview ↗

Response to Lbgd 2/2

We also test our methods on classical RL Games like mazes. Its action is state-dependent and advantages are computed by backward dynamic programming. The results is reproduced from Appendix D, Table 10 in the revised manuscript:

MapHorizonRawELVER-AffineBox-unboundedELVER-BoxUniform
Looped rooms640.006550.006410.005620.005620.98900
Looped rooms1280.022160.021950.017170.016581.05093
Looped rooms2560.155440.154710.131810.086440.94701
Staggered gates640.001710.001690.001600.001601.04037
Staggered gates1280.021290.020970.014660.012740.88099
Staggered gates2560.054180.053860.048640.047120.92775
Four rooms640.005430.005310.004350.004351.04434
Four rooms1280.032550.032180.026900.025610.91857
Four rooms2561.041281.038691.007940.623971.10421

The two experiments support that

  • The Box method can provide good approximation of exact advantages under a Good teacher. It may be under-perfomed to the Uniform method with the guidance of a Bad teacher. So the approximation is determined by the teacher quality, which support our above discussion that the HCA theory support exact advantage reconstruction but biased teacher may miss it.
  • The Goal III is important. We remove the box constraint (Box-unbounded), and the performance decay.

The more detailed information can be seen in the Appendix C and D of revised manuscript.

Question 1. Comparisons with OPDVR, RLSD, and CSCR

We have addressed the missing OPDVR comparison by adding the experiment described under Weakness 1, together with results from repeated training runs. We also added the Box-unbounded ablation and the two exact-advantage RL experiments to examine the reconstruction mechanism. The revised PDF includes the OPDVR and Box-unbounded results in Table 2 and the RL reconstruction experiments in Appendices C and D.

RLSD and CSCR are relevant additional baselines. Due to the available compute budget and the time constraints of the rebuttal period, we have not been able to complete their training and evaluation. We choose the new baseline comparison on OPDVR, which directly combines the teacher and verifier information used in our setting.

Question 2. Is ELVER a purely heuristic credit assignment method?

As we give a detailed discussion in Weakness 2 part, ELVER would give approximation to the real advantage function affected by teacher quality. Our added two classical RL experiments support this, which report the approximation may be nteed by the quality of teacher (Good or Bad). As we discussed, the approximation to exact advantage function is guaranteed by the HCA theory coming from the Bayesian recursion. Our method is to properly use the biased teacher evidence to reconstruct the approximated advantages under reasonable constraints.

Thanks for the authors' response.

  1. Regarding the experiment, the authors add OPDVR as a baseline, but RLSD and CSCR are not run due to time constraint. While the reason is acceptable, the baselines are necessary as they are closely related to the proposed method.
  2. This concern is resolved.

Given the missing baselines in experiments, I will keep the score.

Thank you for the review.

Baselines

RLSD: seeing the paper of RLCSD[1], we choose RLCSD other than RLSD since the performance comparison there, the performance of RLCSD is reported in the first draft. And in the first rebuttal round we think to add RLSD is low-ranked.

CSCR[2]: CSCR does not publish thier original code yet. So we do not add.

RLCSD[1]: RLCSD: Reinforcement learning with contrastive on-policy self-distillation. arXiv preprint arXiv:2606.11709, 2026.

CSCR[2]: Not all tokens deserve equal credit: Counterfactual sensitivity credit reallocation for long-CoT reasoning. arXiv preprint arXiv:2607.27888

Reviewer_5psBOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

The ELVER study looks at methods for turning possibly biased feedback from local teachers into token-level credits that are in line with the final verification results. It treats the allocation of credits as a process of reconstructing the value path over the whole reasoning pathway, and links the teacher's evidence to the final outcome by means of endpoint correction or through joint reconstruction subject to constraints on the probability range. The experiments were carried out under two fixed teacher scenarios and one self-distillation scenario, using five mathematical reasoning benchmarks: AMC23, AIME24, AIME25, AIME26, and HMMT-Feb26.

Critical strengths

The process of formalizing the paper is closely linked to the design of the algorithm. In the case of the Box reconstruction problem, it offers a guarantee of uniqueness, a numerical solution, and an analysis of the reconstruction error. The experiments looked at the final performance under two fixed teacher setups and one self-distillation setup, and also included comparisons between Raw/Affine/Box, synthetic error responses, solution iterations, and a time analysis, thus supporting the practical training value of constrained reconstruction in the settings that were tested.

Critical weaknesses
  1. The reliability of actual teacher evidence still lacks sufficient verification. Even if the overall ability of teachers is strong, it does not mean that the likelihood ratio they provide for each reasoning prefix is close to the actual hindsight ratio. Although the main text acknowledges that teacher preferences and styles may introduce biases, it has not yet verified the gap between actual teacher evidence and the distribution of success conditions, as well as the impact of these gaps on credit reconstruction.
  2. Meeting the structural constraints does not mean that the local credit is accurate. Fixing the endpoints and restricting the intermediate value to [0,1][0,1] still cannot uniquely determine the true intermediate success probability. The unique solution of Box is determined jointly by the given evidence and the fitting rules, so it may also fit a structurally legal but locally incorrect path. The reconstruction error bound still depends on the initial value error, evidence mismatch, and curvature factors, and cannot independently prove that Box is closer to the true advantage than other estimation methods.
  3. The independent contribution of probability range constraints has not been fully isolated. Raw, Affine, and Box not only use different constraints but also adopt different reconstruction methods. The existing comparisons can support the effectiveness of the complete Box scheme, but lack a control group that maintains the same fitting goal and endpoints, and only removes the internal [0,1][0,1] constraint. Therefore, it is still not possible to clearly distinguish the benefits brought by the range constraints and the overall fitting method separately.
  4. Synthetic error experiments cannot replace the local credit verification in real reasoning. Controlled Gaussian evidence noise and initial value deviation experiments support error analysis in specific synthetic settings, but the manuscript has not verified through independent continuation estimation whether the reconstructed value is close to the success probability of students under the real prefix, nor has it systematically examined teacher evidence that satisfies the constraints structurally but has locally incorrect judgments. Therefore, there is still a lack of direct experimental connection between the improvement in final task performance and the more accurate local credit estimation.
Questions for authors

See weaknesses.

4 comments
AuthorsOpenReview ↗

Response to 5psB 1/2

Thank you for distinguishing structural consistency from accurate local credit, and for identifying the need to validate teacher evidence and isolate the contribution of probability bounds. We have added two RL experiments with exact student advantage references and a Box-unbounded ablation to the revised manuscript.

Weakness 1. Reliability of teacher evidence and its effect on credit reconstruction

Successful-trajectory fine-tuning provides a learning-based motivation for the teacher evidence. Supervised fine-tuning (SFT) on verified successful completions trains a model to imitate the token choices made along those trajectories. Russo [1] formalizes this connection: for trajectories generated by a fixed behavior policy π\pi, the success-conditioned policy minimizes the population next-token prediction loss on successful trajectories,

\mathbb E_{\tau\sim\pi(\cdot\mid R=1)} \left[-\sum_t\log q(y_t\mid s_t)\right], \qquad q_{+,t}(y)=\pi(y\mid s_t,R=1).$$ It implies that, the finetuned LLM chosen as the teacher may provide the approximated hindsight evidence. **Our maze experiment implements this successful-trajectory training mechanism directly.** In Appendix D of revised manuscript, we freeze a student policy, sample its trajectories, choose successful trajectories, and fit a teacher to their state–action pairs. We then test whether the learned teacher evidence allows Box to reconstruct the exact student advantages. **Appendix D, Table 9** reports decreases of Box's relative advantage errors as the number of chosen successful trajectories $N_+$ increases. | $N_+$ | $T=64$ | $T=128$ | $T=256$ | | ---: | ---: | ---: | ---: | | 128 | 2.24212 | 4.20227 | 13.59798 | | 1,024 | 1.00682 | 2.84149 | 10.99637 | | 8,192 | 0.26351 | 1.13431 | 6.08444 | | 65,536 | 0.05247 | 0.24218 | 1.74605 | | 1,048,576 | **0.00383** | **0.01804** | **0.18901** | | Uniform | 0.97497 | 1.01051 | 1.09862 | We could see that after $N_+$ is large enough, the relative advantage errors would be less than one, meaning that the Box method is approximating the exact advantages. These results may support the proposed mechanism: **The finetuned (LLM) teacher approximates the required success-conditioned distribution, and sufficiently informative evidence enables Box to accurately reconstruct the student's advantages.** [1] Daniel J. Russo. [Success Conditioning as Policy Improvement: The Optimization Problem Solved by Imitating Success](https://arxiv.org/abs/2601.18175). ICML, 2026. # Weakness 2. Approximating true advantages from biased teacher evidence **Our aim is to properly use biased teacher evidence to approximate the student's true advantages.** Computing exact token advantages throughout LLM training is generally impractical, motivating estimates based on the available evidence. The Hindsight Credit Assignment identity in Proposition 1 connects success-conditioned evidence to the true advantage. As discussed under Weakness 1, a teacher can approximate this evidence. Our focus is therefore on using it effectively together with the observed verifier outcome and appropriate constraints. Our three design goals guide this approximation. Endpoint consistency incorporates the verifier's global credit budget, uniform credit specifies the allocation when teacher evidence provides no local discrimination, and probability bounds keep the reconstructed values within the range of success probabilities. Box fits the teacher evidence subject to these requirements. Theorem 3 bounds the resulting advantage error in terms of optimization error, initial-value error, and evidence mismatch, with sensitivity determined by curvature. To evaluate this approximation directly, we added **two RL experiments that compare the estimated credits with exact student advantages**, reported in Appendices C and D of the revised manuscript. Both experiments use the exact initial value and measure normalized total advantage error, where lower is better. **Majority voting.** A student generates binary actions and receives a terminal reward when a strict majority are ones. Exact values and advantages are available from binomial probabilities, allowing us to evaluate approximation accuracy under both Good and Bad teachers. The following results reproduce **Appendix C, Table 7** in revised version: | Horizon | Teacher | Raw | ELVER-Affine | Box-unbounded | ELVER-Box | Uniform | | ---: | --- | ---: | ---: | ---: | ---: | ---: | | 32 | Good | 0.9696 | 0.9393 | 1.0570 | **0.5528** | 0.9688 | | 128 | Good | 1.1556 | 1.1466 | 1.1751 | **0.6297** | 0.9922 | | 512 | Good | 1.2531 | 1.2507 | 1.1252 | **0.5535** | 0.9980 | | 1024 | Good | 1.2821 | 1.2809 | 1.1301 | **0.6046** | 0.9990 | | 32 | Bad | 3.3653 | 3.2601 | 3.4494 | 2.7892 | **0.9688** | | 128 | Bad | 3.7068 | 3.6779 | 3.8958 | 3.1397 | **0.9922** | | 512 | Bad | 3.8909 | 3.8833 | 3.9269 | 3.1159 | **0.9980** | | 1024 | Bad | 3.9465 | 3.9426 | 3.9961 | 3.1535 | **0.9990** |
AuthorsOpenReview ↗

Response to 5psB 2/2

Maze environments. We evaluate three mazes with state-dependent student policies, whose exact advantages are computed by backward dynamic programming. Teachers are fitted to successful student trajectories as described under Weakness 1. The following results from Appendix D, Table 10 compare all five methods, using the teachers trained with N+=1,048,576N_+=1{,}048{,}576 successful trajectories:

MapHorizonRawELVER-AffineBox-unboundedELVER-BoxUniform
Looped rooms640.006550.006410.005620.005620.98900
Looped rooms1280.022160.021950.017170.016581.05093
Looped rooms2560.155440.154710.131810.086440.94701
Staggered gates640.001710.001690.001600.001601.04037
Staggered gates1280.021290.020970.014660.012740.88099
Staggered gates2560.054180.053860.048640.047120.92775
Four rooms640.005430.005310.004350.004351.04434
Four rooms1280.032550.032180.026900.025610.91857
Four rooms2561.041281.038691.007940.623971.10421

These experiments show that ELVER-Box approximates the true advantages more accurately when teacher evidence is informative. With the Good teacher in the majority task and the learned teachers in the maze experiments, Box achieves normalized errors below one and lower mean errors than Raw, Affine, and Uniform across the reported settings. With the Bad teacher, Uniform performs better, showing that approximation accuracy depends on evidence quality. These comparisons directly support our objective of using biased teacher evidence to approximate true advantages.

Full experimental details are provided in Appendices C and D of the revised manuscript.

Weakness 3. Isolating the contribution of probability bounds

Same as the Question 2 of Reviewer ViK1, we have discussed Box-unbounded, in Section 4.3 and Table 2. It retains the normalized least-squares objective Φ\Phi in Eq. (14), the teacher evidence, and both fixed endpoints, and removes only the internal probability bounds. We compare the two methods under the DeepSeek-R1-Distill-Qwen-1.5B setting. The following table report the results with three training seeds

MethodAMC 2023AIME 2024AIME 2025AIME 2026HMMT Feb. 2026Avg.
Box-unbounded75.06 ± 0.1933.23 ± 1.0332.92 ± 0.5933.44 ± 1.0319.22 ± 0.5438.77 ± 0.68
ELVER-Box80.60 ± 0.2836.70 ± 0.8434.37 ± 0.8935.31 ± 0.9619.29 ± 0.7141.26 ± 0.49

The exact-advantage experiments showed in Weakness 2 also isolate this contribution. Box has lower advantage error than Box-unbounded in all experiments. Therefore, all of the experimental results support the key contribution of probability bounds.

Weakness 4. Direct local-credit validation beyond synthetic perturbations

Independent Monte Carlo evaluation of real LLM prefixes requires many additional student continuations and could not be completed within the available compute and time budget. To directly assess local credit accuracy, we added two RL experiments that compare reconstructed advantages with the student's exact advantages, as described under Weakness 2 and in Appendices C and D of the revised manuscript.

The majority task provides analytic advantages and tests both Good and Bad teachers. The maze experiments use teachers learned from successful student trajectories, with exact advantages computed independently by backward dynamic programming. These experiments evaluate approximation under prescribed or learned teacher evidence. The results under Weakness 2 show that Box approximates true advantages more accurately when the evidence is informative, while the Bad-teacher results expose inaccurate local credit despite structural feasibility.

Thank you for the detailed response from the author, as well as the new Box-unbounded ablation, multi-seed results, and two synthetic experiments with exact advantages. The comparison between Box-unbounded and Box basically answers my question about the original W3. However, these three-seed results were not included in the revised version, and Table 2 is still a single run. The following core issues remain unresolved:

1. The reliability of teacher evidence (original W1). The argument based on success-conditioning in the reply requires the teacher to fit on the current student's successful trajectories, as is the case in the maze experiment. However, the paper actually uses fixed teachers trained independently and self-teachers with privileged information, which do not approach the q+q_+ of the current student, and q+q_+ changes with training. Therefore, this argument does not cover the actual setting of the paper. Moreover, Table 9 shows that even if the teacher directly fits the student's successful trajectories, with T=256T = 256 and N+=65,536N_+ = 65{,}536, the error is 1.75, which is higher than 1.10 of Uniform, and approximately 10610^6 trajectories are needed to reduce it to 0.19. And the row with N+=1,048,576N_+ = 1{,}048{,}576 is marked as a post-result extension (added after seeing the results). The required data grows rapidly with the horizon. These results are unfavorable evidence for the transfer to real LLM settings.

2. Structural feasibility does not equal local accuracy (original W2). Under the Bad teacher, the error of Box is three times that of Uniform. The author admits that this is "inaccurate local credit despite structural feasibility". The bound of Theorem 3 depends on evidence mismatch, but this quantity has never been measured on a real teacher, and the method does not have a mechanism to identify bad teachers. Section 4 of the revised version only states that "its improvement over Uniform depends on teacher evidence quality", without explaining that Box may be approximately 3 times worse than Uniform under bad teachers. The conclusion does not discuss the limitations.

3. The connection between advantage accuracy and final performance (original W4). The MC validation on real LLM prefixes has not yet been provided. This validation only needs to be conducted on a subset: for example, 200–300 prefixes, each with 32 continuations, approximately 10,000 continuations in total, which is equivalent to the rollouts of approximately 40 training steps (256 rollouts per step), less than 4% of one 1,000-step training run. However, the synthetic experiments used by the author to replace it are inconsistent with the LLM results: in the Good teacher setting of the majority task, Raw and Box-unbounded have normalized advantage errors equal to or worse than Uniform at all horizons. That is to say, according to the author's own metrics, the advantage estimates of these two methods are not more accurate than uniform credit allocation (i.e., GRPO). However, in the LLM training (Table 2, DeepSeek-R1-Distill-Qwen-1.5B), the two methods respectively outperformed GRPO by 7.50 and 10.47 points (35.32, 38.29 vs. 27.82), which is much greater than the 3.53 points that ELVER-Box had over Box-unbounded. If the synthetic settings can represent the situation of LLM, then most of the improvement on LLM cannot be attributed to more accurate advantage estimation, but is more likely to come from the teacher signal itself; if they do not represent, then it cannot replace the validation on real LLM prefixes.

Based on above points, i will keep my score.

Thank you for your careful review. Since we do not have enough time and compute source for every experiment with multi-seeds we only show the results with multi-seeds in the review.

The reliability of teacher evidence (original W1).

teacher choosing: the reviewer query the mismatch of different teacher choosing of maze experiment and the actual LLM setting. Since the successful trajectories cannot be obtained from human experience, we just take from students, SFT is to obtain the higher performance model as the teacher. And based on our estimator, the success probability of trained teacher report in the following table, we could see its sucess rate is high enough with increasing data size, corresponding to the comman sense that high success rate model can be chosen as a teacher

N+N_+Looped roomsStaggered gatesFour rooms
12893.18123%93.27631%96.91318%
1,02498.05497%98.15551%98.45448%
8,19299.57160%99.66466%99.62099%
65,53699.93121%99.94711%99.92679%
73,72899.93847%99.95267%99.93339%
131,07299.96461%99.97197%99.95933%
1,048,57699.99543%99.99620%99.99404%
Student76.45259%73.11266%93.66783%

Therefore based on our view, in LLM and maze we alwasy choose the higher performance model to be the teacher. For majority tasks, the good teacher is obtained by priori setting with higher probs actting 1, it is not based on student trajectories but has the same performance like "higher success rate" as maze experiments. Base on this view (simiar as the discussion in W2 how to identify teacher), we think the majorty and maze results can provide support for actual LLM setting.

As for self-teacher, it is based on the sense that privileged information can provide guidance, which may be the basis for self-distillation, i.e., we approximate success-conditioning probability π(a∣s,R=1)\pi(a\mid s, R=1) with π(a∣s,privileged information)\pi(a\mid s, \text{privileged information}), where the model can self-guide its way according to the useful information (like answer, some hints).

Moreover, we startup a quick validation for MC in real LLM setting, please see the newest our response to reviewer Vik1.

incresing data size: we think the increasing data size for obtaining a good teacher actually reveal the data scaling law for training a good model, the credit error suppots that. Here data size is not the problem of efficiency. Therefore, in the LLM setting, we choose the well-post-trained teacher for the student model. Btw, we test more cases of N+N_+ which is the extended results of table 9 in the revised version, please see the following table, we increase N+N_+ about 4 times from 65k ->266k, the error reduce around 1/3 (H:64 0.05->0.019, H128:0.242->0.073, H256 1.74->0.60), in the case of 266k the Box has obtained the lower normalized credit error than Uniform for all horizon cases.

Teacher budget N+N_+H=64H=128H=256
1282.242124.2022713.59798
1,0241.006822.8414910.99637
8,1920.263511.134316.08444
65,5360.052470.242181.74605
73,7280.046310.220881.64974
131,0720.035500.136241.10215
262,1440.019940.073310.59942
1,048,5760.003830.018040.18901
Uniform0.974971.010511.09862

Structural feasibility does not equal local accuracy (original W2).

We admmit your query. The identification of Bad teacher may be out of scope in this work. In the actual LLM domain, the most effiecient way to identify good or bad teacher is to see their performance on different benchmarks. Based on the theory of Russo's paper, we choose the well-post-trained model based on the student model in the same domain. The writting in the revised version may get confused, we do not avoid mentioning the bad performance of Box on bad teacher, it is reasonable based on the quality of teacher. We would address these limitation in the future.

The connection between advantage accuracy and final performance (original W4).

As above mentioned, please see our response to reviewer Vik1.

In our synthetic results, the majority tasks show that Raw, Affine may behave worse than Uniform, the maze tasks show that Raw, Affine behave better than Uniform (N=1048kN_=1048k), and for Raw, Affine methods even Box, their performance depends on the teacher signal, that is our startup point. In the first response we say ** ELVER-Box approximates the true advantages more accurately when teacher evidence is informative.**, when teacher signal is strong, Raw and Affine could help, but they may not obey the Goal II and Goal III in our design, then we derive Box who meets all, whose performance exceeds them. Based on our scope, the work of direct exact performance comparison from classical RL to LLM RL, which always acts like idea-guidance.

Reviewer_Vik1OpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper studies token-level credit assignment in RLVR by combining teacher-guided on-policy distillation signals with trajectory-level verification rewards. It uses teacher–student token likelihood ratios as a proxy for changes in eventual success probability and defines token credits as differences between adjacent prefix values. ELVER-Affine applies a uniform correction to enforce the trajectory’s total credit budget, while ELVER-Box jointly reconstructs the value path using teacher signals and verifier rewards, with fixed endpoints and intermediate values constrained to [0,1].

Critical strengths
  1. The constrained reconstruction formulation is coherent: teacher signals guide local transitions, while endpoint conditions and probability bounds constrain the overall value path.
  2. Box obtains favorable point estimates across the tested settings, providing preliminary evidence that joint reconstruction can improve on the evaluated alternatives.
Critical weaknesses
  1. The methodological contribution is insufficiently isolated and validated. Likelihood-ratio value recursion and the total credit budget overlap with OPPO [1]. Box changes both the objective and constraints relative to Affine, leaving the specific benefit of the [0,1] bounds unclear. The theory establishes properties of the reconstruction problem, but does not establish more accurate values or advantages. Independent validation against Monte Carlo prefix values and an ablation removing only the intermediate bounds would strengthen the central claim.

  2. The experiments do not establish a reliable practical advantage over strong, information-matched baselines. OPPO [1] and OPDVR [2] are absent, while comparisons with GRPO and OPD respectively introduce teacher information and verifier supervision. The modest gains over stronger evaluated baselines lack training-seed variability. Moreover, the serial solver estimate is approximately 30.8% of rollout time, without measured end-to-end overhead or matched-compute comparisons. Figure 3(b) mixes per-batch rollout time with per-trajectory solver time, making the practical cost difficult to assess.

[1] Li, Yu, et al. “OPPO: Bayesian Value Recursion for Token-Level Credit Assignment in LLM Reasoning.” arXiv:2605.21851, 2026.

[2] Lin, Wenze, et al. “On-policy Distillation with Verifiable Reward.” arXiv:2608.24696, 2026.

Questions for authors
  1. What evidence shows that Box reconstructs more accurate prefix values or token advantages? Could this be evaluated against independent Monte Carlo estimates on representative trajectories?
  2. How does Box perform when only the intermediate [0,1] constraints are removed, while retaining the objective in Eq. (14) and both fixed endpoints?
  3. Could the authors provide comparisons with OPPO and OPDVR under the same teacher and verifier information, together with variation across training seeds?
  4. What is the measured end-to-end training overhead, including teacher scoring and reconstruction? Do the gains persist under matched compute budgets? Please report rollout and solver times separately.
3 comments
AuthorsOpenReview ↗

Response to ViK1 1/3

Thank you for identifying the comparisons needed to assess the contribution: direct validation of local credit, an ablation that isolates probability bounds, and comparisons with additional baselines. We have added exact-ground-truth reconstruction experiments, the Box-unbounded ablation, and an OPDVR comparison in the revised manuscript.

Weakness 1. Isolation and validation of the methodological contribution

Our likelihood-ratio formulation builds on return-conditioned HCA [3]. The endpoint telescoping identity is a standard consequence of summing successive value differences. Related constructions appear in the telescoping sum of temporal-difference residuals in GAE [4] and the return decomposition through consecutive Q-value differences in RUDDER [5].

There is a specific issue in identifying the evidence implemented in OPPO [1] with the evidence required by its exact recursion. Let q+(y)=π(y∣s,R=1)q_+(y)=\pi(y\mid s,R=1), q−(y)=π(y∣s,R=0)q_-(y)=\pi(y\mid s,R=0), v=π(R=1∣s)v=\pi(R=1\mid s), and p(y)=vq+(y)+(1−v)q−(y)p(y)=vq_+(y)+(1-v)q_-(y). Eq. (10)-(12) admit an exact log-odds update requiring the success-to-failure Bayes factor q+(y)/q−(y)q_+(y)/q_-(y). However, OPPO incorrectly substitutes the marginal token probability p(y)p(y) for the failure-conditioned token probability q−(y)q_-(y). Since these probabilities are generally different, this substitution invalidates the claimed exact log-odds update.

In our method, Affine is the simplest try to recover the credit under endpoint consistency and Bayesian recursion. But in our experiments, it show no improvement. So we focus on how to propose a proper algorithm motivated by the uniform credit allocation. The [0,1][0,1] bounds derive from the probability bounds of values under un-discounted sparse reward RL setting. It would provide legal value reconstruction guidance.

Our additional experiments show its key role (see detail discussion in the following answers to Question 1 and 2). Since estimating the exact advantages of long trajectories of LLM is hard due to the computational source and time limit, we conduct two classical RL experiments, which show that our methods recover the more accurate advantage functions theoretically guaranteed by the HCA theory. The three Goals are designed how to properly use the biased teacher evidence. The effort of Box method is mainly decrease the biased ineffect on reconstruction.

[3] Anna Harutyunyan et al. Hindsight Credit Assignment. NeurIPS, 2019.

[4] John Schulman et al. High-Dimensional Continuous Control Using Generalized Advantage Estimation. ICLR, 2016.

[5] Jose A. Arjona-Medina et al. RUDDER: Return Decomposition for Delayed Rewards. NeurIPS, 2019.

Weakness 2. Practical advantage, baselines, training variability, and computational cost

For OPPO, it has significant theoretical distinction discussed in Weakness 1 and it does not publish their original code yet, so we do not choose them as our additional baseline. We report OPDVR's results in Deepseek-R1-Distill-Qwen-1.5B setting with three training seeds in the following discussion of Question 3. The computational cost estimation may cause confusing, we give a detailed discussion in Question 4.

AuthorsOpenReview ↗

Response to Vik1 2/3

Question 1. Evidence for more accurate prefix values or token advantages

Since independent Monte-Carlo evaluation on LLM prefixes is hard due to the compute and time budget, we have added two RL experiments that compare reconstructed advantages directly with the student's exact advantages.

Firstly, based our theory, HCA provides the identity linking success-conditioned action probabilities to the student's Bellman values. With exact evidence and the exact initial value, this identity recovers the true advantages. Our method focus on how to properly use the biased teacher evidence to reconstruct the most approximated advantages. With good estimator of values, Theorem 3 states that the Box method would recover the true advantages.

Majority votes. Secondly, we conduct the simple majority experiments. A student generates binary actions and receives a terminal reward if a strict majority are ones. Exact values and advantages follow from binomial probabilities. We evaluate both Good and Bad teachers. The following results report normalized total advantage error (Appendix C, Table 7 in revised version):

HorizonTeacherRawELVER-AffineBox-unboundedELVER-BoxUniform
32Good0.96960.93931.05700.55280.9688
128Good1.15561.14661.17510.62970.9922
512Good1.25311.25071.12520.55350.9980
1024Good1.28211.28091.13010.60460.9990
32Bad3.36533.26013.44942.78920.9688
128Bad3.70683.67793.89583.13970.9922
512Bad3.89093.88333.92693.11590.9980
1024Bad3.94653.94263.99613.15350.9990

Maze environments. We also evaluate three mazes, with exact student advantages computed by backward dynamic programming. Teachers are learned from successful student trajectories. The table reproduces results in Appendix D (Table 10):

MapHorizonRawELVER-AffineBox-unboundedELVER-BoxUniform
Looped rooms640.006550.006410.005620.005620.98900
Looped rooms1280.022160.021950.017170.016581.05093
Looped rooms2560.155440.154710.131810.086440.94701
Staggered gates640.001710.001690.001600.001601.04037
Staggered gates1280.021290.020970.014660.012740.88099
Staggered gates2560.054180.053860.048640.047120.92775
Four rooms640.005430.005310.004350.004351.04434
Four rooms1280.032550.032180.026900.025610.91857
Four rooms2561.041281.038691.007940.623971.10421

These experiments show that: Box reconstructs more accurate advantages when teacher evidence is informative. The ELVER-BOX obtains relative errors less than 1 based on the Good teacher for each experiment setting, showing that it approximate the true advantages. With the Bad teacher, Uniform performs better, showing that reconstruction accuracy depends on evidence quality.

Full experimental details are provided in Appendices C and D of the revised manuscript.

Question 2. Removing only the intermediate probability bounds

We have added exactly this control, named Box-unbounded, in Section 4.3 and Table 2 of revised manuscript. It solves

=argmin_{\substack{v_{2:T}\in\mathbb R^{T-1}\;v_1=\widehat V_1^{\pi}\;v_{T+1}=R}} \Phi(v)$$ using the same normalized least-squares objective $\Phi$ from Eq. (14), teacher evidence, and fixed endpoints as Box. Its internal values solve $Hv^{\mathrm{unb}}=d$. In the discussion of Question 1, we report results of the Box-unbounded method, which remove the intermediate $[0,1]$ constraints, its behavior is under-performed by the Box method which has the constraints. So the results show the key contribution of probability bounds. We also test Box-unbounded method with three training seeds. The following table report the mean-std accuracy for additional OPDVR method and Box-unbounded method. | Method | AMC 2023 | AIME 2024 | AIME 2025 | AIME 2026 | HMMT Feb. 2026 | Avg. | | --- | ---: | ---: | ---: | ---: | ---: | ---: | | OPDVR | 66.25 ± 0.71 | 22.29 ± 0.44 | 24.90 ± 0.00 | 23.49 ± 1.70 | 13.97 ± 0.47 | 30.18 ± 0.48 | | Box-unbounded | 75.06 ± 0.19 | 33.23 ± 1.03 | 32.92 ± 0.59 | 33.44 ± 1.03 | 19.22 ± 0.54 | 38.77 ± 0.68 | | **Box** | **80.60 ± 0.28** | **36.70 ± 0.84** | **34.37 ± 0.89** | **35.31 ± 0.96** | **19.29 ± 0.71** | **41.26 ± 0.49** | As we can see **Box** method surpasses the **Box-unbounded** method. The evidence therefore supports a contribution from the probability bounds. We have included the experiment result in the revised manuscript with additional reward and response length reported. See Section 5.
AuthorsOpenReview ↗

Response to Vik1 3/3

Question 3. Information-matched baselines, training variability, and the relation to OPPO

In the above discussion, we choose add OPDVR and Box-unbounded with three training seeds and report them in the discussion of Question 2. Because OPPO has theoretical distinction and does not publish their code yet, considering the compute and time budget, we do not compare it.

The results show that the Box method still outperforms other methods and OPDVR may have little help for the case of thinking models. More detailed information is reported in the revised manuscript.

Question 4. Computational overhead and matched compute

We agree that the original Figure 3(b) mixed per-trajectory and per-step timings, obscuring the computational cost. We have revised the figure to use seconds per training step throughout. Since each trajectory can be reconstructed independently, we have also updated the practical code to use parallel workers.

The following table reproduces results from Figure 3(b). The number of rollout trajectories is 32×8=25632\times 8=256, we use 16 parallel workers for advantage reconstruction of Box method.

Component16-worker projection (s/step)Percentage (%)
Rollout, including teacher scoring73.8740.24
Student log-probability computation25.0913.67
Advantage construction1.760.96
Actor update79.4143.26
Weight synchronization and other step work3.431.87
Total training step183.56100.00

We could see that the Rollout and Actor update time consume 83% timing cost, the Advantage construction only accounts for 0.96%. This indicates that reconstruction can occupy a small fraction of training time since trajectories are processed in parallel. However, we could gain much more validation accuracy improvement compared to other RL methods, which practically show the efficiency of ELVER-Box.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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