- Rating
- 2(+1)
- Confidence
- 2
- Informativeness
- 2
- Presentation
- 1
- Soundness
- 2
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Paper summary
This paper studies causal-effect estimation under unobserved confounding. The authors adopt the proxy causal learning framework in which two observed proxies carry complementary information about a latent confounder. They propose DR-PCL-NET, a doubly robust neural estimator that learns two bridges, one from the treatment side and one from the outcome side, and combines them so that error in either bridge is mitigated by the other. Their treatment bridge requires no density-ratio estimation, a step that burdens earlier methods, and a single bridge fit serves all subgroup and heterogeneous queries. The paper further establishes nonasymptotic projected error bounds showing that the doubly robust error is governed by the smaller of the two bridge errors rather than by a separate density-ratio term. The authors stress-test each bridge route in isolation and then evaluate on benchmarks that include continuous treatments and image-valued structured treatments. Across these settings DR-PCL-NET attains the best or near-best causal mean squared error relative to single-bridge and fixed-kernel baselines.
Critical strengths
1、It removes the density-ratio estimation bottleneck and extends proxy causal learning to continuous and image-valued treatments.
2、Its doubly robust estimator is provably governed by the smaller bridge error and yields all three response types from a single fit.
Critical weaknesses
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The presentation is difficult to follow, with an overloaded formula-heavy main text, an identification argument that is hard to trace, and figures too small to read, which makes the contributions hard to assess.
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The nonasymptotic bounds are stated only for approximate empirical minimizers, whereas the estimator is trained by a nonconvex stochastic procedure whose convergence the authors explicitly leave open, so the theory does not certify the algorithm behind the reported results.
Questions for authors
1、Please remake the figures with legible text, as the current text is difficult to read. The writing and figure-drawing skills require improvement.
2、The guarantees hold for approximate empirical minimizers, while the method is trained by a nonconvex stochastic procedure without a convergence result. Can you report the optimization error actually attained on the reported benchmarks and compare it with the MSE gaps between your method and the baselines, so the empirical support for the theory becomes visible?
3、Since the submission cites but never compares Bingxi Zhang, Tao Shen, and Yifan Cui. Neural estimation of treatment bridge functions for proximal causal inference. Statistical Analysis and Data Mining: An ASA Data Science Journal, 18(5): e70045, 2025. doi: https://doi.org/10.1002/sam.70045.the closest neural treatment-bridge estimator.
3 comments
Thank you for the reply. The DeepMMR comparison answers my question, and I am glad to see TreatmentNet wins in three of the four settings. The Natality study and the ablations are also real work, I appreciate them. I also read your explanation about the optimization question, I will not push it further.
My main complaint is still the presentation. Enlarging the fonts helps, but the real problem is not the font size. The main text is still one formula after another, and there is still no figure that gives an overview of the framework, how the pieces are connected and where the final estimators come from. To be honest, the figure problem in the submitted version is something one careful read by the authors themselves would find. As I wrote in the review, the writing and the figures need more care. So my suggestion is simple: continue to polish the paper, the writing, the figures, and add one roadmap figure of the whole framework. The method may be good, but the current form makes the reader work too hard to see it.
With the new evidence from the rebuttal, I raise my score from 1 to 2. I hope the authors continue improving the manuscript.
Thank you for reconsidering your assessment. We are glad that the new DeepMMR comparison answered your question, and we appreciate your positive feedback on the Natality study and the ablations. During the rebuttal, we initially focused on the additional experiments you and the other reviewers requested.
To address your concern about presentation, we have now added Figures 2 and 3 and Algorithm 1 to Section 4. Figure 2 shows the treatment and outcome bridges side by side and points to the losses used to learn each one. Figure 3 shows how we combine the two bridges to obtain a doubly robust estimate of the population dose-response. We weight the OutcomeNet residuals with the treatment bridge, regress them on dose, and add the fitted correction to the outcome-bridge average. Algorithm 1 brings these steps together in pseudocode so readers can see how to obtain the final estimate at a given dose. In the final version, we will further refine these figures and use them to guide readers through the overall algorithm and the derivation of the estimators.
In light of these revisions, we would be grateful if you would consider raising your recommendation to accept.
Thank you for your review. We aim to address each of your concerns and questions below as well as in the updated manuscript. We are happy to provide further clarifications if needed. If our revisions and responses resolve your concerns, we would appreciate it if you would increase your score.
We enlarged the fonts and graphical elements in Figures 1–2 and the fonts in Tables 1–2. To make identification easier to follow, Section 3 now explains the roles of target-specific reweighting, doubly robust residual correction, and conditional normalization, through which one population bridge serves heterogeneous response targets. We welcome specific pointers to any remaining steps that would benefit from clarification.
We hope these revisions make the connection between our identification results, estimators, and statistical guarantees clearer. Together, these contributions provide a framework for population, heterogeneous, and treatment-conditional response estimation under continuous or structured treatments. Under the stated assumptions, our projected-error analysis establishes causal-response consistency without requiring strong L2 convergence of either bridge.
Our bounds quantify how statistical, approximation, and optimization errors affect causal estimation. They are conditional on approximate empirical minimization; we do not claim a global convergence guarantee for the implemented alternating neural optimizer. Section 5 and Theorem 5.1 retain the optimization terms, and the limitations identify optimizer convergence as an open problem.
For example, Chen et al. (2025) establish optimization guarantees for two-layer non-parametric instrumental variable regression (NPIV) networks using a dedicated bilevel mean-field Langevin algorithm with entropy and quadratic regularization. Their analysis suggests a direction for developing optimization guarantees for our method, which is why we cite it when discussing future work. Extending these ideas to our deeper architectures and alternating updates would constitute a much more general and open research problem than the reduced scope of our present statistical analysis for our proxy causal learning problem. Our bounds explicitly quantify how the achieved optimization accuracy affects the statistical error.
Regarding the requested empirical gap, Assumption H.1 requires approximate empirical minimization at each stage:
Rj(ϑj)≤infϑ∈VjRj(ϑ)+ξj.
The global infimum is unknown, so training or validation loss cannot be reported as the attained global optimization gap. Moreover, bridge objectives are not causal MSE: their optimization errors must be propagated through the statistical bound, rather than compared directly with MSE differences between methods. Remark H.44 specifies the optimization accuracy sufficient to preserve the statistical rates.
Zhang et al. study neural treatment-bridge estimation for binary treatments, whereas our main contribution targets continuous and structured treatment spaces. Since binary treatment is a special case of our framework, we added a direct comparison of TreatmentNet with DeepMMR-U and DeepMMR-V on their S1 and S4 designs at n∈{2,000,4,000}. We use the authors' released DGPs, DeepMMR training code, and per-arm configurations.
All methods use a common 75% fit/25% validation split and an independent test sample of 1,000. We compute ATE MSE as (ATE−ATE)2, average three repetitions within each of ten data-generating seeds, and report the mean ± standard error across seed means.
TreatmentNet achieves the lowest mean ATE MSE in three of four settings. At n=4000, it outperforms both DeepMMR variants in mean ATE MSE on both designs. The comparison, DGPs, and experimental protocol are included in Appendix I.8, Table 8, of the revised manuscript.