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Paper summary
This paper proposes ER-LVR, a probabilistic extension of latent visual reasoning that replaces deterministic latent embedding alignment with a stochastic prediction head trained using an energy-score objective. The authors argue that conventional MSE-based alignment does not adequately represent the residual mismatch between generated visual thoughts and their target visual embeddings. The paper establishes a relationship between the energy-score exponent, mean alignment, and latent dispersion, showing that the learned scale follows the alignment residual under specific assumptions. Empirical evaluations on spatial planning, out-of-domain visual understanding, and paired semantic queries demonstrate improvements over representative latent reasoning baselines. Additional controlled experiments investigate the predicted latent geometry and the effects of policy optimization.
Critical strengths
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The paper offers a focused and mathematically motivated improvement to latent visual reasoning. Instead of introducing a large collection of architectural modifications, ER-LVR identifies a specific limitation of deterministic representation alignment and studies it through a probabilistic objective. The analysis of the energy-score boundary and the conditional scale optimum provides a clear mechanism with testable predictions.
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The controlled objective comparisons are particularly valuable. The experiments distinguish deterministic MSE alignment, stochastic per-sample MSE, mean-matching alignment, and the proposed energy objective. The geometry measurements are also connected directly to the theoretical predictions. This makes the contribution more convincing than a simple demonstration that adding stochasticity improves downstream accuracy.
Critical weaknesses
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The interpretation of learned dispersion as uncertainty or reliability requires more careful qualification. The key relation between dispersion and alignment residual is derived under fixed-center, isotropic, and high-dimensional concentration assumptions. Moreover, the deterministic-target result implies that the unrestricted optimum has zero dispersion. Consequently, learned scale may primarily reflect representation mismatch or optimization error rather than calibrated uncertainty about visual evidence. The paper does not sufficiently establish that the dispersion provides a reliable measure of downstream prediction correctness or perceptual ambiguity.
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The practical role of stochastic latent states at inference remains insufficiently isolated. Several principal evaluations use deterministic inference with zero sampling noise and averaged latent predictions. The reported accuracy gains therefore support the effectiveness of the training objective, but do not necessarily establish that modeling or propagating uncertainty improves reasoning at inference time. In addition, the main policy optimization results suggest that most additional RL gains arise from the text policy rather than adaptation of the stochastic latent head.
Questions for authors
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Does the learned dispersion correlate with downstream correctness, perceptual ambiguity, or sensitivity to visual perturbations on held-out examples? Calibration plots or risk-coverage measurements would help clarify whether the scale is useful beyond matching the alignment residual.
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How robust is the predicted residual-dispersion relation when the isotropy and high-dimensional concentration assumptions are violated? Can the authors provide diagnostics of directional covariance, anisotropy, or per-example residual-scale correlation rather than primarily aggregate measurements?
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Can the authors compare deterministic mean decoding, stochastic decoding, and uncertainty-aware latent aggregation under matched computational budgets? This would clarify whether ER-LVR is primarily a better training regularizer or an uncertainty-aware reasoning mechanism.
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What is the empirical sensitivity to the energy-score exponent and the number of stochastic samples, and how does the additional computation compare with deterministic LVR under an equal training budget?
5 comments
Response to Reviewer YjY3 — Part 2: Correctness and residual–spread diagnostics
Q1 — Dispersion and downstream correctness. We evaluated whether larger learned spread predicts answer errors on held-out or validation examples. Each question is scored by its mean spread across latent steps, an aggregation fixed in advance. For this diagnostic, answers are generated with the mean of K=8 latent draws at σ=1, matching the Stage-1 training feed rather than the zero-noise setting of the main benchmarks.
| Training lineage | Evaluation set | ER-LVR AUROC | Squared-error control AUROC (same head) |
|---|---|---|---|
| Visual-CoT | Held-out V*, 115 questions | 0.316 | 0.365 |
| VSP | Validation, 100 questions (seed 42) | 0.539 | 0.251 |
| Zebra-CoT Jigsaw | Held-out V*, 56 questions that emitted a latent span | 0.567 | 0.367 |
These point estimates do not support using larger dispersion as a reliable answer-error score across the evaluated settings. The Jigsaw result is conditional on the 56 of 115 questions that emitted a latent span. Our theory concerns embedding alignment residuals, not downstream correctness; Appendix D leaves that relationship open. We have not evaluated perceptual ambiguity or sensitivity to visual perturbations and will clarify this scope in the revision.
Q2 — Robustness and per-example diagnostics. We address this through per-example analyses of both the objective’s conditional optimum and the trained head’s realized spread, reported in our response to Reviewer o6QR (W1a and Q1).
The held-out diagnostic holds each predicted centre fixed and directly minimizes the energy score over the scale of its empirical sample cloud. It neither imposes isotropy nor substitutes the concentration approximation. The optimal radius closely tracks the alignment residual (slope 1.042; Pearson 0.983), with essentially the same slope when the residual is estimated from an independent cloud (1.043).
The trained head shows a weaker positive association on held-out examples (Pearson 0.200, 95% CI [0.060, 0.330]). The association also replicates across three VSP training seeds, as reported in o6QR’s Q1; these VSP measurements are in-distribution.
These diagnostics provide the requested per-example evidence and support the conditional prediction’s empirical applicability on the evaluated geometries. They distinguish the trained head’s partial realization from the objective’s optimum, without establishing isotropy or robustness to arbitrary assumption violations. Proposition 2 retains its stated assumptions.
Response to Reviewer YjY3 — Part 3: Aggregation, sensitivity and computation
Q3 — Decoding and dispersion-aware aggregation. We added a dispersion-aware aggregation experiment alongside the deterministic and stochastic decoding comparison reported to Reviewer hy1Q (Q1a).
Using the Table 6 checkpoint and self-consistency protocol, we generated eight chains per question at σ=1, with four latent steps. We saved each chain’s answer and per-step spread without altering generation, then compared unweighted majority vote with a vote weighted by the inverse of each chain’s mean spread. The weighting rule was fixed before evaluation and tests whether lower spread identifies more reliable chains; it is not a component of ER-LVR.
Both voting rules reuse identical chains and spread measurements, giving them the same generation budget. Weighting requires no additional model generation.
| Aggregation over the same eight chains | V* (%) | MMVP (%) |
|---|---|---|
| Unweighted majority vote | 81.68 | 73.33 |
| Dispersion-weighted vote | 81.68 | 73.00 |
The chains are unanimous on 190 of 191 V* questions and 294 of 300 MMVP questions, leaving only seven questions where the voting rules could differ. Dispersion weighting changes one answer, from correct to incorrect, and does not improve on majority vote at the same generation budget.
For comparison, the one-pass evaluations reported to Reviewer hy1Q (Q1a) give 82.20% on V* across deterministic, single-draw and mean-of-eight decoding; MMVP varies from 73.00% to 73.33%. Those modes share the latent-step budget but differ in head-evaluation count, whereas the aggregation experiment uses eight generation passes.
The reported performance is therefore available with deterministic latent decoding. The tested sampling and aggregation procedures show no consistent additional benefit in these evaluations. We position ER-LVR’s demonstrated benefit around energy-based training, rather than an established uncertainty-aware inference mechanism, and will clarify this scope in the revision.
Q4a — Exponent and sample count. The Visual-CoT objective ablation (Table 6) varies α with the head, target and data held fixed:
| Exponent | V* accuracy (%) | MMVP accuracy (%) | rep/fid |
|---|---|---|---|
| α=1 | 82.20 | 73.00 | 0.946 |
| α=2 boundary | 80.63 | 70.67 | 0.177 |
The α=1 arm scores higher on both benchmarks and has an aggregate spread ratio closer to the predicted landmark.
We additionally ran an exploratory, single-seed VSP sweep, starting each arm from the same checkpoint (seed 42). Each arm changes only α or K, keeping β=3.33, 2,500 optimizer steps and eight latent steps fixed. Evaluation uses greedy text decoding and σ=0 on the same 100 validation examples.
| Configuration | Validation accuracy (%) | End-of-training rep/fid |
|---|---|---|
| α=1, K=8 — default | 77 | 1.007 |
| α=1.5, K=8 | 78 | 0.999 |
| α=2, K=8 — boundary | 76 | 0.240 |
| α=1, K=4 | 77 | 1.006 |
| α=1, K=16 | 74 | 1.008 |
Each variant is within three correct answers of the default. The aggregate geometry is more distinct: α=1 and α=1.5 yield ratios near one, consistent with Proposition 2’s α-independent conditional optimum under its stated assumptions. The α=2 boundary, which has no preferred spread under Proposition 1, remains below that landmark in this experiment.
The ratio also remains near one across K=4, 8 and 16. At a fixed context and predictive distribution, equation 6 is unbiased for each tested K, although changing K can affect optimization and the fed sample mean. These measurements support the predicted scale behavior without establishing downstream superiority for a particular α or K.
Q4b — Computation relative to deterministic LVR. Increasing K repeats head evaluations, not backbone evaluations; the energy objective adds target distances and pairwise sample distances.
We timed both methods under the Table 6 recipe on the same H200 node using 40-step runs. Measurements span completion of step 1 to completion of step 40, covering 39 optimizer-step intervals:
| Method | Elapsed time over 39 intervals | Mean time per interval |
|---|---|---|
| Deterministic LVR | 3,152 s | 80.82 s |
| ER-LVR, K=8 | 3,130 s | 80.26 s |
The observed difference is approximately 0.7%, indicating comparable training throughput at an equal number of optimizer steps in this measurement.
At σ=0, all K draws coincide, so inference can use one head evaluation per latent step—the same head network and evaluation count as the deterministic LVR baseline.
Response to Reviewer YjY3 — Part 1: Interpretation and inference
We thank the reviewer for recognizing the focused theoretical contribution and the value of the controlled objective comparisons. We address the interpretation of dispersion and the scope of our evidence below.
W1a — Dispersion reflects alignment mismatch, not calibrated uncertainty. Our analysis characterizes the dispersion scale selected by the energy objective in relation to representation mismatch. The alignment residual b is the distance between the predicted centre and its target embedding; under its stated assumptions, Proposition 2 identifies the energy-minimizing scale at a fixed centre as equal to this residual. The held-out diagnostics reported in our response to Reviewer o6QR (Part 1, W1a) support this conditional prediction and show positive, though weaker, residual-dependent modulation in the trained head. We will clarify this scope and remove wording that could suggest calibrated uncertainty about visual evidence.
W1b — The assumptions and the zero-dispersion optimum. Proposition 2 retains its fixed-centre, isotropy and concentration assumptions. The empirical rescaling diagnostic reported to Reviewer o6QR (W1a) supports its conditional prediction on the evaluated geometries without imposing isotropy or the concentration approximation; it does not verify those assumptions.
Proposition 3 and §2.4 state that the unrestricted optimum for a deterministic target is the point mass at that target. This is compatible with Proposition 2: under its assumptions, a centre constrained away from the target has a nonzero optimal radius, which approaches zero as the alignment residual vanishes. The trained head realizes this conditional relationship only partially, as the same diagnostics show.
W1c — Downstream correctness and perceptual ambiguity. As detailed in our answer on downstream correctness, the evaluated settings do not support using larger spread as a reliable answer-error score. This distinguishes its association with embedding alignment residuals from downstream reliability. We will report this limitation explicitly. Whether a dedicated training signal can make spread useful for correctness prediction, and whether it reflects perceptual ambiguity or sensitivity to visual perturbations, remain directions for future work.
W2a — ER-LVR is a training-time method. ER-LVR’s reported gains are obtained after energy-based training and with deterministic latent decoding. The comparison reported to Reviewer hy1Q (Q1a) shows identical V* accuracy across zero-noise, single-draw and mean-of-eight decoding, with MMVP differing by one answer out of 300. This comparison fixes the latent-step budget, not the number of head evaluations.
Essentially the same observed performance is available with one deterministic head evaluation per latent step. Table 6’s self-consistency comparison likewise shows no consistent improvement. We do not claim an additional inference-time benefit from propagating uncertainty. We will clarify this scope and replace “the mechanism trained is the mechanism deployed” with the precise statement that the trained head is used on the decode path.
W2b — RL gains come from the text policy. The reviewer’s observation matches our finding: GRPO and Energy-GRPO improve the supervised ER-LVR starting points by 1.89 and 2.06 points on average, respectively, with positive gains in all three seeds (Table 5). This demonstrates that policy optimization can improve a latent-reasoning model within our framework. For context, Table 1 reports a decline after GRPO for the vanilla SFT baseline (59.17 → 55.33).
Continuing to train the noise tilt adds 0.17 points on average, but this difference changes sign across seeds and lies within seed variation (§4). We therefore identify text-policy optimization as the established source of the RL improvement and will distinguish it from the unestablished additional benefit of tilt adaptation in the contributions.