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Under review as a conference paper at ICLR 2027

ER-LVR: RESIDUAL-ADAPTIVE DISPERSION FOR LATENT VISUAL REASONING

Abstract

Latent visual reasoning lets a vision–language model reason over visual evidence without first translating it into words: at designated positions it outputs a continu- ous hidden state in place of a token and feeds it back as the next input embedding. Existing methods train these visual thoughts by regressing each such state onto a target embedding from the model’s own frozen vision encoder. In practice the alignment is imperfect, and the error that remains reflects how well a particular vi- sual thought was formed, yet a single vector carries no trace of it: a visual thought that missed its target re-enters the model’s reasoning looking exactly like one that hit. We show that this is a property of the objective. Squared-error alignment is the degenerate boundary of the energy-score family, at which the score constrains only the mean of the predicted distribution; in the strictly proper interior the scale is constrained as well, and at the optimum it equals the distance from the distribu- tion’s mean to the target, so the spread of a visual thought tracks its own alignment error. We instantiate this as ER-LVR, which replaces the deterministic alignment head with a reparameterized stochastic head trained under an energy objective, and verify that the learned geometry converges to the predicted landmark while two control objectives sharing the same head do not. On spatial planning ER-LVR exceeds the strongest prior latent method by 2.3 points, and by 3.2 with policy optimization of the text policy; it matches or exceeds every latent baseline on out- of-domain visual understanding, and improves joint accuracy on paired semantic queries over a same-backbone baseline.

Primary area:
applications to computer vision, audio, language, and other modalities
Keywords:
multimodal large language models, vision Language Models, multimodal reasoning

Reviews

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1234this paper, Top 49%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.33 over 3 reviews, above 51% of the others.
Reviewer_YjY3OpenReview ↗
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3
Confidence
2
Informativeness
3
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Paper summary

This paper proposes ER-LVR, a probabilistic extension of latent visual reasoning that replaces deterministic latent embedding alignment with a stochastic prediction head trained using an energy-score objective. The authors argue that conventional MSE-based alignment does not adequately represent the residual mismatch between generated visual thoughts and their target visual embeddings. The paper establishes a relationship between the energy-score exponent, mean alignment, and latent dispersion, showing that the learned scale follows the alignment residual under specific assumptions. Empirical evaluations on spatial planning, out-of-domain visual understanding, and paired semantic queries demonstrate improvements over representative latent reasoning baselines. Additional controlled experiments investigate the predicted latent geometry and the effects of policy optimization.

Critical strengths
  1. The paper offers a focused and mathematically motivated improvement to latent visual reasoning. Instead of introducing a large collection of architectural modifications, ER-LVR identifies a specific limitation of deterministic representation alignment and studies it through a probabilistic objective. The analysis of the energy-score boundary and the conditional scale optimum provides a clear mechanism with testable predictions.

  2. The controlled objective comparisons are particularly valuable. The experiments distinguish deterministic MSE alignment, stochastic per-sample MSE, mean-matching alignment, and the proposed energy objective. The geometry measurements are also connected directly to the theoretical predictions. This makes the contribution more convincing than a simple demonstration that adding stochasticity improves downstream accuracy.

Critical weaknesses
  1. The interpretation of learned dispersion as uncertainty or reliability requires more careful qualification. The key relation between dispersion and alignment residual is derived under fixed-center, isotropic, and high-dimensional concentration assumptions. Moreover, the deterministic-target result implies that the unrestricted optimum has zero dispersion. Consequently, learned scale may primarily reflect representation mismatch or optimization error rather than calibrated uncertainty about visual evidence. The paper does not sufficiently establish that the dispersion provides a reliable measure of downstream prediction correctness or perceptual ambiguity.

  2. The practical role of stochastic latent states at inference remains insufficiently isolated. Several principal evaluations use deterministic inference with zero sampling noise and averaged latent predictions. The reported accuracy gains therefore support the effectiveness of the training objective, but do not necessarily establish that modeling or propagating uncertainty improves reasoning at inference time. In addition, the main policy optimization results suggest that most additional RL gains arise from the text policy rather than adaptation of the stochastic latent head.

Questions for authors
  1. Does the learned dispersion correlate with downstream correctness, perceptual ambiguity, or sensitivity to visual perturbations on held-out examples? Calibration plots or risk-coverage measurements would help clarify whether the scale is useful beyond matching the alignment residual.

  2. How robust is the predicted residual-dispersion relation when the isotropy and high-dimensional concentration assumptions are violated? Can the authors provide diagnostics of directional covariance, anisotropy, or per-example residual-scale correlation rather than primarily aggregate measurements?

  3. Can the authors compare deterministic mean decoding, stochastic decoding, and uncertainty-aware latent aggregation under matched computational budgets? This would clarify whether ER-LVR is primarily a better training regularizer or an uncertainty-aware reasoning mechanism.

  4. What is the empirical sensitivity to the energy-score exponent and the number of stochastic samples, and how does the additional computation compare with deterministic LVR under an equal training budget?

5 comments
AuthorsOpenReview ↗

Response to Reviewer YjY3 — Part 1: Interpretation and inference

We thank the reviewer for recognizing the focused theoretical contribution and the value of the controlled objective comparisons. We address the interpretation of dispersion and the scope of our evidence below.

W1a — Dispersion reflects alignment mismatch, not calibrated uncertainty. Our analysis characterizes the dispersion scale selected by the energy objective in relation to representation mismatch. The alignment residual b is the distance between the predicted centre and its target embedding; under its stated assumptions, Proposition 2 identifies the energy-minimizing scale at a fixed centre as equal to this residual. The held-out diagnostics reported in our response to Reviewer o6QR (Part 1, W1a) support this conditional prediction and show positive, though weaker, residual-dependent modulation in the trained head. We will clarify this scope and remove wording that could suggest calibrated uncertainty about visual evidence.

W1b — The assumptions and the zero-dispersion optimum. Proposition 2 retains its fixed-centre, isotropy and concentration assumptions. The empirical rescaling diagnostic reported to Reviewer o6QR (W1a) supports its conditional prediction on the evaluated geometries without imposing isotropy or the concentration approximation; it does not verify those assumptions.

Proposition 3 and §2.4 state that the unrestricted optimum for a deterministic target is the point mass at that target. This is compatible with Proposition 2: under its assumptions, a centre constrained away from the target has a nonzero optimal radius, which approaches zero as the alignment residual vanishes. The trained head realizes this conditional relationship only partially, as the same diagnostics show.

W1c — Downstream correctness and perceptual ambiguity. As detailed in our answer on downstream correctness, the evaluated settings do not support using larger spread as a reliable answer-error score. This distinguishes its association with embedding alignment residuals from downstream reliability. We will report this limitation explicitly. Whether a dedicated training signal can make spread useful for correctness prediction, and whether it reflects perceptual ambiguity or sensitivity to visual perturbations, remain directions for future work.

W2a — ER-LVR is a training-time method. ER-LVR’s reported gains are obtained after energy-based training and with deterministic latent decoding. The comparison reported to Reviewer hy1Q (Q1a) shows identical V* accuracy across zero-noise, single-draw and mean-of-eight decoding, with MMVP differing by one answer out of 300. This comparison fixes the latent-step budget, not the number of head evaluations.

Essentially the same observed performance is available with one deterministic head evaluation per latent step. Table 6’s self-consistency comparison likewise shows no consistent improvement. We do not claim an additional inference-time benefit from propagating uncertainty. We will clarify this scope and replace “the mechanism trained is the mechanism deployed” with the precise statement that the trained head is used on the decode path.

W2b — RL gains come from the text policy. The reviewer’s observation matches our finding: GRPO and Energy-GRPO improve the supervised ER-LVR starting points by 1.89 and 2.06 points on average, respectively, with positive gains in all three seeds (Table 5). This demonstrates that policy optimization can improve a latent-reasoning model within our framework. For context, Table 1 reports a decline after GRPO for the vanilla SFT baseline (59.17 → 55.33).

Continuing to train the noise tilt adds 0.17 points on average, but this difference changes sign across seeds and lies within seed variation (§4). We therefore identify text-policy optimization as the established source of the RL improvement and will distinguish it from the unestablished additional benefit of tilt adaptation in the contributions.

AuthorsOpenReview ↗

Response to Reviewer YjY3 — Part 2: Correctness and residual–spread diagnostics

Q1 — Dispersion and downstream correctness. We evaluated whether larger learned spread predicts answer errors on held-out or validation examples. Each question is scored by its mean spread across latent steps, an aggregation fixed in advance. For this diagnostic, answers are generated with the mean of K=8 latent draws at σ=1, matching the Stage-1 training feed rather than the zero-noise setting of the main benchmarks.

Training lineageEvaluation setER-LVR AUROCSquared-error control AUROC (same head)
Visual-CoTHeld-out V*, 115 questions0.3160.365
VSPValidation, 100 questions (seed 42)0.5390.251
Zebra-CoT JigsawHeld-out V*, 56 questions that emitted a latent span0.5670.367

These point estimates do not support using larger dispersion as a reliable answer-error score across the evaluated settings. The Jigsaw result is conditional on the 56 of 115 questions that emitted a latent span. Our theory concerns embedding alignment residuals, not downstream correctness; Appendix D leaves that relationship open. We have not evaluated perceptual ambiguity or sensitivity to visual perturbations and will clarify this scope in the revision.

Q2 — Robustness and per-example diagnostics. We address this through per-example analyses of both the objective’s conditional optimum and the trained head’s realized spread, reported in our response to Reviewer o6QR (W1a and Q1).

The held-out diagnostic holds each predicted centre fixed and directly minimizes the energy score over the scale of its empirical sample cloud. It neither imposes isotropy nor substitutes the concentration approximation. The optimal radius closely tracks the alignment residual (slope 1.042; Pearson 0.983), with essentially the same slope when the residual is estimated from an independent cloud (1.043).

The trained head shows a weaker positive association on held-out examples (Pearson 0.200, 95% CI [0.060, 0.330]). The association also replicates across three VSP training seeds, as reported in o6QR’s Q1; these VSP measurements are in-distribution.

These diagnostics provide the requested per-example evidence and support the conditional prediction’s empirical applicability on the evaluated geometries. They distinguish the trained head’s partial realization from the objective’s optimum, without establishing isotropy or robustness to arbitrary assumption violations. Proposition 2 retains its stated assumptions.

AuthorsOpenReview ↗

Response to Reviewer YjY3 — Part 3: Aggregation, sensitivity and computation

Q3 — Decoding and dispersion-aware aggregation. We added a dispersion-aware aggregation experiment alongside the deterministic and stochastic decoding comparison reported to Reviewer hy1Q (Q1a).

Using the Table 6 checkpoint and self-consistency protocol, we generated eight chains per question at σ=1, with four latent steps. We saved each chain’s answer and per-step spread without altering generation, then compared unweighted majority vote with a vote weighted by the inverse of each chain’s mean spread. The weighting rule was fixed before evaluation and tests whether lower spread identifies more reliable chains; it is not a component of ER-LVR.

Both voting rules reuse identical chains and spread measurements, giving them the same generation budget. Weighting requires no additional model generation.

Aggregation over the same eight chainsV* (%)MMVP (%)
Unweighted majority vote81.6873.33
Dispersion-weighted vote81.6873.00

The chains are unanimous on 190 of 191 V* questions and 294 of 300 MMVP questions, leaving only seven questions where the voting rules could differ. Dispersion weighting changes one answer, from correct to incorrect, and does not improve on majority vote at the same generation budget.

For comparison, the one-pass evaluations reported to Reviewer hy1Q (Q1a) give 82.20% on V* across deterministic, single-draw and mean-of-eight decoding; MMVP varies from 73.00% to 73.33%. Those modes share the latent-step budget but differ in head-evaluation count, whereas the aggregation experiment uses eight generation passes.

The reported performance is therefore available with deterministic latent decoding. The tested sampling and aggregation procedures show no consistent additional benefit in these evaluations. We position ER-LVR’s demonstrated benefit around energy-based training, rather than an established uncertainty-aware inference mechanism, and will clarify this scope in the revision.

Q4a — Exponent and sample count. The Visual-CoT objective ablation (Table 6) varies α with the head, target and data held fixed:

ExponentV* accuracy (%)MMVP accuracy (%)rep/fid
α=182.2073.000.946
α=2 boundary80.6370.670.177

The α=1 arm scores higher on both benchmarks and has an aggregate spread ratio closer to the predicted landmark.

We additionally ran an exploratory, single-seed VSP sweep, starting each arm from the same checkpoint (seed 42). Each arm changes only α or K, keeping β=3.33, 2,500 optimizer steps and eight latent steps fixed. Evaluation uses greedy text decoding and σ=0 on the same 100 validation examples.

ConfigurationValidation accuracy (%)End-of-training rep/fid
α=1, K=8 — default771.007
α=1.5, K=8780.999
α=2, K=8 — boundary760.240
α=1, K=4771.006
α=1, K=16741.008

Each variant is within three correct answers of the default. The aggregate geometry is more distinct: α=1 and α=1.5 yield ratios near one, consistent with Proposition 2’s α-independent conditional optimum under its stated assumptions. The α=2 boundary, which has no preferred spread under Proposition 1, remains below that landmark in this experiment.

The ratio also remains near one across K=4, 8 and 16. At a fixed context and predictive distribution, equation 6 is unbiased for each tested K, although changing K can affect optimization and the fed sample mean. These measurements support the predicted scale behavior without establishing downstream superiority for a particular α or K.

Q4b — Computation relative to deterministic LVR. Increasing K repeats head evaluations, not backbone evaluations; the energy objective adds target distances and pairwise sample distances.

We timed both methods under the Table 6 recipe on the same H200 node using 40-step runs. Measurements span completion of step 1 to completion of step 40, covering 39 optimizer-step intervals:

MethodElapsed time over 39 intervalsMean time per interval
Deterministic LVR3,152 s80.82 s
ER-LVR, K=83,130 s80.26 s

The observed difference is approximately 0.7%, indicating comparable training throughput at an equal number of optimizer steps in this measurement.

At σ=0, all K draws coincide, so inference can use one head evaluation per latent step—the same head network and evaluation count as the deterministic LVR baseline.

Reviewer_o6QROpenReview ↗
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Informativeness
2
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Paper summary

This paper proposes ER-LVR for latent visual reasoning in vision–language models. It trains a stochastic latent head with an energy score against frozen visual features. Under fixed-centre, isotropic concentration assumptions, the analysis links optimal distribution scale to alignment residuals. Training combines this objective with next-token prediction, while Energy-GRPO extends the method to policy optimization. Experiments across visual reasoning tasks, supported by geometric diagnostics and ablations, suggest that the method is effective.

Critical strengths
  1. The paper addresses a meaningful problem by studying how training objectives affect the distribution geometry of latent visual representations.

  2. The theoretical analysis is clear and provides useful insights into the relationship between alignment residuals and optimal distribution scale.

  3. Experiments across multiple visual reasoning tasks, together with geometric diagnostics and ablations, show promising results.

Critical weaknesses
  1. The core residual-adaptive dispersion mechanism lacks direct validation. Aggregate statistics do not establish the proposed per-instance relationship, and its contribution to downstream performance remains unclear, especially under deterministic inference.
  2. The independent benefit of the Energy Score remains uncertain. The Stochastic Head alone provides substantial gains, while Energy Score and MSE have different auxiliary gradient strengths.
  3. The Stochastic Head and Energy Score largely follow CALM, limiting methodological novelty.
Questions for authors
  1. Does latent spread track per-example alignment residuals, and how does this information contribute to reasoning during deterministic inference?
  2. Does Energy Score still outperform MSE when auxiliary gradient strength is matched or the MSE weight is tuned?
4 comments
AuthorsOpenReview ↗

Response to Reviewer o6QR — Part 1: Mechanism and objective contribution

We thank the reviewer for recognizing the theoretical analysis, geometric diagnostics and results across visual reasoning tasks. We address the concerns below with new held-out diagnostics and controlled comparisons.

W1a — The per-instance relation, now tested directly.

We evaluate 115 held-out V* direct-attribute examples, with no matching image basenames in the Visual-CoT SFT corpus. Targets use the same construction function as training. Four latent steps yield 460 item–step measurements; confidence intervals resample whole examples with their four steps kept together.

The trained energy head exhibits a positive association between spread and alignment residual:

Trained headPearson correlation95% CI
Energy0.200[0.060, 0.330]
Squared-error control, identical architecture0.013[−0.129, 0.158]

We separately test Proposition 2’s conditional prediction by holding each predicted centre fixed, rescaling its sample cloud, and directly minimizing the energy score over scale:

MeasurementResult
Optimal-radius versus residual slope1.042, 95% CI [1.010, 1.070]
Pearson correlation0.983
Slope using an independent cloud to estimate the residual1.043

These results support the approximate conditional scale prediction on the evaluated geometries without imposing isotropy in the diagnostic. The independent-cloud result indicates that the relationship is not driven by reuse of the same draws.

The trained head realizes weaker modulation than the conditional optimum: its spread–residual slope is 0.015, the median optimal rescaling is 2.0, and 97.6% of item–step pairs favor increasing spread. We will distinguish the positive trained association from attainment of the optimum.

W1b — Contribution under deterministic inference. A training-time effect does not require stochastic sampling at deployment. Our noise controls, reported in the response to Reviewer hy1Q (Q1a–Q1b), are evaluated with σ=0 and greedy text decoding. Adding calibrated training noise improves the MSE control on V* but lowers MMVP accuracy; energy remains numerically ahead.

The inference comparison likewise shows essentially the same performance with or without latent sampling: V* remains 82.20%, while MMVP varies by one answer out of 300. The full decoding table appears in that response.

Together, these results provide direct per-example evidence for residual-dependent spread and compare the training controls under deterministic deployment. They distinguish these findings from the stronger causal claim that residual-dependent modulation itself accounts for the accuracy gains.

W2 — Independent benefit of the Energy Score. Table 6 separates deterministic and stochastic head operation from the choice of alignment objective. To assess the Energy Score’s additional contribution, we compare it directly with a reweighted MSE control using the same stochastic head.

Section 4 reports auxiliary-to-next-token gradient-norm ratios of 2.72 for energy and 1.05 for MSE. Using these ratios, we increased the MSE coefficient from β=0.1 to β=0.259. The two arms use the same head architecture, initialization, data, seed and learning-rate schedule, and are evaluated under the Table 6 protocol:

MethodV* accuracy (%)MMVP accuracy (%)
Reweighted squared error, β=0.25978.5372.67
ER-LVR, Energy Score, β=0.182.2073.00

Under this reweighting, energy retains a 3.67-point V advantage*, while the MMVP difference is 0.33 points, or one answer out of 300. Increasing the MSE weight therefore does not reproduce the energy arm’s V* result in this controlled comparison. We will distinguish this observed advantage from a claim of superiority across all benchmarks or MSE weights.

AuthorsOpenReview ↗

Response to Reviewer o6QR — Part 2: CALM and author questions

W3 — Relationship to CALM. CALM and ER-LVR share the use of a stochastic head and the energy score; our contribution concerns the objective’s role in a different setting. CALM predicts compressed text vectors, with training targets sampled from a learned Gaussian posterior, and decodes predicted vectors into text for feedback. ER-LVR instead aligns intermediate visual reasoning states to deterministic embeddings from a frozen vision encoder and feeds the resulting latents directly into the reasoning process.

This setting motivates our conditional scale analysis. Under the stated fixed-centre, isotropy and concentration assumptions, the energy objective selects a radius equal to the remaining alignment residual. We distinguish this result from both the spread-indifferent α=2 boundary and the unrestricted deterministic-target optimum, which collapses at the target. Our held-out ER-LVR diagnostic supports the conditional prediction on actual latent geometries (optimal-radius versus residual slope 1.042; Pearson correlation 0.983), while showing that the trained head realizes it only partially.

Our controlled experiments evaluate these consequences within ER-LVR. Figure 3 compares sensitivity to latent-span removal with the head architecture held fixed, while Table 6 and the reweighted-MSE comparison assess the alignment objective’s additional contribution. Our contribution is the conditional scale analysis and its empirical evaluation in latent visual reasoning; we do not claim novelty for the stochastic head or energy score themselves.

Q1 — Per-example alignment and deterministic inference. Yes, the trained energy head shows a positive per-example residual–spread association, although its modulation is substantially weaker than the objective’s conditional optimum.

As detailed in W1a, on 115 held-out V* examples, the trained head’s spread correlates positively with the alignment residual: Pearson 0.200, 95% CI [0.060, 0.330], compared with 0.013 [−0.129, 0.158] for the squared-error control. Separately, the fixed-centre optimal radius closely tracks the residual (slope 1.042, Pearson 0.983); estimating the residual from an independent sample cloud gives essentially the same slope (1.043).

The trained association also replicates on VSP training examples across three seeds: energy-head Pearson correlations are 0.501, 0.534 and 0.551, compared with 0.057, −0.059 and −0.036 for the squared-error control. These VSP measurements are in-distribution; the V* measurements above provide the held-out evidence.

Under deterministic latent decoding (σ=0), the K head outputs coincide, so sampled dispersion is not directly supplied to the decoder. As reported in W1b, varying latent decoding between zero noise, a single stochastic draw and the mean of K=8 draws leaves V* accuracy at 82.20%, with MMVP accuracies of 73.00%, 73.33% and 73.33%, respectively.

These results establish a positive residual–spread association and show that essentially the same observed performance is available under deterministic latent decoding. The training controls in W1b assess the objective’s contribution under that deployment setting; they do not establish that residual-dependent modulation itself causes the accuracy gains. We will distinguish these findings explicitly.

Q2 — Comparison with reweighted MSE. We tested two squared-error weights with the stochastic head, both trained with the same initialization, data and settings as the Table 6 model and evaluated under the Table 6 protocol. The first uses the Energy Score’s weight, β=0.1 (Table 6). The second is a reweighted control, β=0.259, which rescales the MSE weight using the auxiliary-to-next-token gradient-norm ratios reported in §4: 2.72 for the Energy Score versus 1.05 for MSE (lines 465–467).

MethodV* accuracy (%)MMVP accuracy (%)
Squared error, β=0.1 — Table 681.1571.67
Reweighted squared error, β=0.25978.5372.67
ER-LVR, Energy Score, β=0.1 — Table 682.2073.00

Neither MSE weight matches the Energy Score on V* (+1.05 and +3.67 points). On MMVP, the margins are +1.33 and +0.33 points, respectively. Increasing the MSE weight lowers V* accuracy and slightly raises MMVP accuracy, so the effect of reweighting is benchmark-dependent. These results show that the Energy Score retains its numerical advantage over both the original and gradient-ratio-informed MSE settings in this comparison.

Dear Reviewer,

Thank you again for your thoughtful review of our submission. We have put considerable time and effort into addressing your comments, including additional analyses and clarifications, and have posted a detailed response.

As the discussion period ends soon, we would be grateful if you could look at our response when you have a moment and consider whether it addresses your concerns. If so, we would kindly ask you to consider updating your assessment.

We are happy to answer any further questions or provide additional clarification.

Best regards, The Authors

AuthorsOpenReview ↗

Follow-up on Per-Example Validation, Objective Controls, and CALM

Dear Reviewer o6QR,

As the discussion deadline approaches, we wanted to briefly follow up. We added held-out per-example diagnostics, comparisons with reweighted MSE and calibrated training noise, and deterministic-inference evaluations. We also clarified our contribution relative to CALM.

The new results support the conditional scale prediction and a positive residual–spread association in the trained head, while energy retains a numerical advantage over both tested MSE weights. We distinguish these findings from a causal explanation of the accuracy gains.

We hope these additions address your concerns and would appreciate hearing whether any questions remain before the deadline. Thank you again for your time.

Best wishes,

The Authors

Reviewer_hy1QOpenReview ↗
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2
Confidence
3
Informativeness
1
Presentation
1
Soundness
2
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Paper summary

The authors argue that in latent visual reasoning models, standard squared-error alignment trains a latent token but underrepresents how far it remains from the visual target. Therefore, they propose ER-LVR, which instead generates a distribution of latent tokens with a stochastic head and trains it with energy scores. Theoretically, the distribution reflects its alignment residual. Experiments show competitive results on several relevant benchmarks.

Critical strengths
  • This paper provides comprehensive experimental results and ablations.
Critical weaknesses
  • The contribution seems incremental, just a component beyond LVR. The improvement seems compositional and rely on textual training. I doubt whether 0.17 points improvement is a substantial improvement, or just random seed noise.
  • The presentation of this paper is problematic. In textual narration, there are a lot typos, like missing the Period in Line 81. Also, the Figure 1 seems having some AI-generated clues, like the white blurs. Besides, "Evaluation and analysis" is not a contribution. At least some findings are required.
Questions for authors
  • Besides, I am wondering whether adding certain random noise into the latent tokens will affect the performance.
4 comments
AuthorsOpenReview ↗

Response to hy1Q — Part 1: Contribution and presentation

We thank the reviewer for the feedback and for recognizing our experimental breadth.

W1a — Contribution. Our contribution analyzes how alignment objectives select latent dispersion. Proposition 1 identifies mean-matching squared error as the α=2 energy-score boundary, which leaves spread unconstrained; per-sample MSE instead penalizes spread. Under its stated assumptions, Proposition 2 identifies the fixed-centre optimal radius as the alignment residual.

The objective also changes sensitivity to latent removal. With the head held fixed, removing the latent span under Figure 3’s protocol costs the energy-trained model 45.7 ± 1.4 MMVP points, versus a change of +1.2 ± 3.9 for the squared-error control.

The empirical improvements are already present after supervised training. CoLVR’s 65.83% on VSP includes its RL stage, while supervised ER-LVR reaches 68.17% without RL (Table 1). Relative to CoLVR’s pre-RL score of 63.50%, the difference is 4.67 points, although the training recipes differ (CoLVR, Table 3).

The out-of-domain and semantic-consistency results are also supervised-only:

  • Out-of-domain (Table 2): ER-LVR matches or exceeds every reported latent baseline on every benchmark 14 of 15 comparisons are positive, with one tie. The largest margins over LVR are +4.53 points on MMStar and +3.53 on CV-Bench.
  • Semantic consistency (Table 3): with the same backbone, training data and alignment targets as LVR, joint accuracy improves by +3.7 points on V*, +2.6 on HR-Bench-4K, and +2.5 on HR-Bench-8K under the shared paired-question protocol.

W1b — Significance. The 0.17-point difference is within seed variation, as §4 (lines 469–472) explicitly states: its sign changes across seeds. The introduction likewise states that continuing to train the noise tilt “adds nothing stable.”

The substantive RL gains are positive across all three paired seeds (Table 5). The supervised starts score 66.50%, 67.83% and 67.00%, each above CoLVR’s reported 65.83%. GRPO improves these starts by +1.83, +2.00 and +1.83 points, and Energy-GRPO by +2.00, +1.67 and +2.50 points. The mean gains are therefore +1.89 and +2.06 points, respectively.

This matters given prior difficulties with RL: CoLVR reports vanilla SFT declining from 59.17 to 55.33 under GRPO, and its own ablation scores 63.50 before RL, 60.33 with normal GRPO, and 65.83 with its latent-trajectory reward (CoLVR, Tables 1 and 3).

Our configuration combines text-policy reward optimization, partial-progress reward shaping and gradient accumulation across problems (§2.6), yielding positive gains in every tested seed. The result is the consistent improvement over the supervised starting point, rather than significance for the additional 0.17-point tilt increment.

W2a — Writing. We corrected line 81 to read “… within seed variation.” We have also proofread the manuscript for similar errors.

W2b — Figure 1. Figure 1 is a conceptual schematic. We replaced the rasterized PNG with a vector PDF to address the visible artifacts and improve clarity. Our AI usage statement discloses LLM assistance with writing and code; responsibility for the manuscript remains ours.

W2c — Contributions. We agree that “Evaluation and analysis” names an activity rather than a finding. We will replace it with three findings:

  1. Latent-span sensitivity: Energy training produces substantially greater sensitivity to latent-span removal than squared-error training with the same head (Fig. 3: −45.7 versus +1.2 percentage points).
  2. Controlled objective comparisons: Controlled comparisons distinguish stochastic-head operation from the alignment objective (Table 6); among the three Table 4 objectives, energy alone yields an aggregate spread ratio near the predicted landmark (1.009 ± 0.003).
  3. Policy optimization: Text-policy RL improves every tested seed, while continued noise-tilt training provides no stable additional gain (Table 5).
AuthorsOpenReview ↗

Response to hy1Q — Part 2: Noise-control experiments

Q1a — Noise at inference has essentially no effect. We evaluated the Table 6 checkpoint with the same evaluation configuration, holding four latent steps:

Latent decodingV* (%)MMVP (%)
Zero-noise point estimate, σ=082.2073.00
Single stochastic draw, σ=182.2073.33
Mean of K=8 draws, σ=182.2073.33

V* accuracy is identical, and MMVP varies by little. Essentially the same observed performance is therefore available with deterministic latent decoding.

Q1b — Noise during training does not reproduce the energy objective’s benefit. We added independent isotropic Gaussian noise after the head to each latent draw of the reweighted MSE control (β=0.259). Its scale, τ=0.433, was calibrated to the energy checkpoint’s measured per-draw dispersion. This placement prevents the head from directly suppressing the injected noise component. The paired MSE controls share initialization, data, objective weight and training schedule, differing only in the added output noise. Evaluation follows the Table 6 protocol:

TrainingV* (%)MMVP (%)
Reweighted MSE, β=0.25978.5372.67
Reweighted MSE + Gaussian noise, τ=0.43381.6871.67
ER-LVR, Energy Score, β=0.182.2073.00

Training noise improves V* but lowers MMVP accuracy. Neither MSE control matches energy’s performance on either benchmark.

Dear Reviewer,

Thank you again for your thoughtful review of our submission. We have put considerable time and effort into addressing your comments, including additional analyses and clarifications, and have posted a detailed response.

As the discussion period ends soon, we would be grateful if you could look at our response when you have a moment and consider whether it addresses your concerns. If so, we would kindly ask you to consider updating your assessment.

We are happy to answer any further questions or provide additional clarification.

Best regards, The Authors

AuthorsOpenReview ↗

Follow-up on Contribution, Presentation, and Noise Controls

Dear Reviewer hy1Q,

As the discussion deadline approaches, we wanted to briefly follow up. Our responses clarify the theoretical contribution and supervised gains independently of the small additional RL increment, address the presentation issues, and provide the requested noise controls during both training and inference.

Together, these clarify that the contribution extends beyond the auxiliary RL result and show that adding noise alone does not reproduce the energy-trained model’s performance in the tested comparisons. We believe these additions address the concerns raised in your review.

We would appreciate hearing whether you agree or whether any questions remain before the deadline. Thank you again for your time.

Best wishes,

The Authors

Comments on the paper

1 comment
AuthorsOpenReview ↗

General Response

We thank the reviewers for their feedback and for recognizing the theoretical analysis and controlled experiments.

During rebuttal, we added:

• Per-example diagnostics: Held-out measurements supporting the conditional scale prediction and showing a positive, weaker residual–spread association in the trained head.

• Objective controls: Reweighted-MSE and calibrated-noise comparisons testing whether auxiliary weighting or added noise explains the observed gains.

• Inference and reliability tests: Deterministic and stochastic latent decoding, dispersion-weighted voting, and held-out correctness measurements.

• Sensitivity and timing tests: Comparisons across energy-score exponents and sample counts, alongside training-time measurements.

In the manuscript, we now distinguish the conditional optimum from what the trained head achieves and clarify that alignment dispersion is not established as calibrated uncertainty. We also replaced “Evaluation and analysis” with concrete findings, corrected presentation issues, and separated the consistent text-policy improvements from the unstable additional noise-tilt gain.

The new results strengthen the evidence for residual-dependent dispersion while making the limits of its downstream interpretation explicit.

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