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- Informativeness
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- Presentation
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Paper summary
The paper proposes RLSR, a reinforcement learning framework that jointly optimizes direct reasoning and multi-turn self-reflection. It uses grouped verifier-guided reflection and zone-of-proximal-development filtering to construct hindsight-conditioned self-teachers. A direct track reshapes step-level advantages using counterfactual likelihood gaps, while a reflection track assigns turn-level rewards through log-odds belief calibration. Experiments on Qwen3-1.7B and Qwen3-4B across mathematics and code generation benchmarks show relatively consistent improvements over several RLVR and self-distillation baselines, with test-time reflection capabilities largely preserved.
Critical strengths
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The paper addresses an important problem: transferring test-time self-correction capabilities into direct policy improvements while preserving reflection ability.
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The framework integrates verifier-guided reflection, hindsight-based credit assignment, and joint optimization in a coherent manner. The evaluation includes diverse baselines, two model scales, multiple benchmarks, and component ablations.
Critical weaknesses
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A fundamental limitation of the direct track: For marginal-ZPD groups where all initial rollouts fail, the GRPO sequence advantage is zero, making the reshaped direct-track advantage identically zero. This contradicts the claimed mechanism for directly internalizing reflection-induced breakthroughs.
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Under-specified reflection credit assignment: The empirical win rate used for log-odds belief updates is insufficiently defined. Single binary outcomes cannot provide meaningful intermediate progress signals, while additional success-rate estimation may require unaccounted rollouts.
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Insufficient grounding and mechanistic ablations: Verifying final outcomes does not validate the causal correctness of generated hindsight, and the ZPD criterion does not always require a successful correction. The ablations also fail to isolate the proposed step-level reshaping and belief-gain mechanisms from ordinary RL objectives.
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Limited novelty and incomplete comparisons: The direct-track design closely resembles the already-evaluated RLSD [2], while turn-level belief calibration and evolving hindsight supervision overlap with AgentOPSD [3] and SEED [4]. The paper also omits discussion of SCoRe [1] and lacks a matched comparison with the cited FlowBalance [5].
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Limited empirical and efficiency evidence: Most improvements over the strongest trained baselines are small, yet the claimed confidence intervals, significance tests, and seed variability are not presented. Matching the maximum rollout count also does not establish comparable total computation given the additional hindsight generation and teacher scoring.
[1] Training Language Models to Self-Correct via Reinforcement Learning
[2] Self-Distilled RLVR
[3] AgentOPSD: Recursive Self-Distillation for Agentic Reinforcement Learning
[4] SEED: Self-Evolving On-Policy Distillation for Agentic Reinforcement Learning
[5] FlowBalance: Verifier-Grounded Self-Improvement from On-Policy Reasoning Experience
Questions for authors
How does the direct track obtain a nonzero learning signal from marginal-ZPD groups when all initial rollouts have zero reward? Resolving this issue is important for assessing the paper's central reflection-to-direct amortization claim.
4 comments
Response to Weakness 3 and Weakness 5
Response to W3: Hindsight grounding, the ZPD criterion, and mechanistic ablations
We agree that verifying a final answer does not verify the causal explanation in its hindsight, and that the original track-level ablations do not isolate the shaping terms. The verifier supplies a successful reference for hindsight generation; the hindsight itself remains model-generated. We will describe it as outcome-anchored supervision and the scoring signal as a hindsight-conditioned likelihood contrast, removing claims of guaranteed causal attribution.
The direct track preserves the sequence advantage's sign and bounds its modification. At the default and , the final multiplier in Eq. (12) lies in , limiting hindsight's influence to a 10% change in step-advantage magnitude. Within-trajectory standardization expresses relative likelihood support among reasoning units. These properties constrain the use of the generated signal; causal correctness would require separate validation.
The reviewer is also correct that Eq. (1) does not require a successful correction in every admitted group. It requires at least one initial failure and at least one verified success among the initial attempts and retries. In a Standard-ZPD group, a successful initial attempt can supply that reference; in a Marginal-ZPD group, admission necessarily requires a successful retry. We will state these two cases explicitly and reserve the failure-to-success description for groups where it occurs.
Common Response C2 addresses the ablation concern with four configurations: full RLSR, removal of direct reshaping, removal of belief gain, and removal of both. Both tracks, their estimators, ZPD filtering, and the training schedule are retained. Removing direct reshaping lowers 4B AIME 2024/2025 by 5.90/2.69 points; removing both terms lowers them by 6.80/3.29 points. Full RLSR has the highest mean on all four reported benchmarks at both scales. These controls support the performance contribution of the shaping terms beyond the plain outcome dual-track objective. They assess that contribution separately from the causal validity of individual hindsights.
Response to W5. Empirical margins, significance, and efficiency
We agree that small margins require explicit uncertainty estimates and that equal maximum rollout counts do not establish equal total computation. Common Response C4 reports measurements over 250 iterations on eight A800 GPUs, including search, verification, hindsight generation, teacher scoring, and optimization. RLSR uses 1.47x/1.62x GRPO's wall-clock time and GPU hours at 1.7B/4B. We will add this profile to the training-cost appendix and describe the protocol as matching maximum trajectory counts, with RLSR's additional training cost quantified separately.
Common Response C5 reports means and sample standard deviations across five independent training runs, paired-instance bootstrap intervals for score differences, and raw two-sided p-values with Holm adjustment across the 16 displayed benchmark-by-scale comparisons. The instance bootstrap averages each problem's scores across the five runs before resampling; its intervals are conditional on those trained models, with seed variability reported separately.
At 4B, RLSR has the highest displayed mean among trained methods on all eight benchmarks. Its gains over the strongest trained baseline on AIME 2025 (+1.98 points) and HMMT 2026 (+2.31 points) remain significant at 0.05 after the stated Holm correction (adjusted p = 0.030 and 0.016). We will distinguish these corrected findings from the remaining numerical margins and add the complete uncertainty results and implemented test definition to the main results and Appendix B.6.
Response to Weakness 4: Novelty justification (1/2)
We thank the reviewer for raising concerns about the novelty and the missing comparison with FlowBalance. RLSR addresses the following question: how can a reasoning model endogenously turn test-time compute—grouped search and sequential self-reflection—into privileged training supervision without an external teacher, a persistent skill repository, or reference-solution context, while preserving reflection ability? Our contribution connects the construction of this supervision to first-attempt learning and explicit retry training. Below, we compare the supervision sources, credit assignment, and optimization objectives of the five related methods.
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RLSD [2]: supervision construction and credit granularity. Both methods preserve verifier-derived update direction and use self-distillation to adjust magnitude. RLSD applies token-level reweighting; RLSR constructs hindsight from verified outcomes in its current search group, aggregates likelihood contrasts into reasoning units, standardizes them within each original attempt, and jointly trains retries. Common Response C3 explains the learning signal for Marginal-ZPD attempts, and C2 isolates the shaping terms. Table 1 reports higher RLSR means than RLSD on all eight benchmarks at both scales, including 74.00 vs. 66.46 on 4B AIME 2024.
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vs. AgentOPSD [3] and SEED [4]: evidence source and hindsight learning. AgentOPSD is also critic-free, using retrieved skills and recursively accumulated teacher–student evidence for turn-level credit. RLSR generates hindsight from its own verified search group and uses a fixed-prior recovery reward, , with temporal credit propagated through discounted returns. SEED already generates evolving on-policy hindsight after an initial skill-SFT stage using external-analyzer annotations. RLSR generates hindsight without that separate initialization and uses it to reshape verifier-derived advantages, while SEED combines outcome RL with a gated auxiliary distillation loss.
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vs. SCoRe [1]: first-attempt amortization and joint training. SCoRe is a relevant precedent: it first trains correction with a strong first-attempt KL constraint, then jointly optimizes both attempts with a progress bonus. RLSR trains original attempts and verifier-gated retries together in one stage, explicitly transferring search-derived hindsight into original-attempt advantages. Its search supports up to retries with early stopping ( here). Table 3 documents retained retry gains alongside first-attempt performance: 4B RLSR improves from 65.09 to 73.33 on AIME 2025 and 50.30 to 55.00 on LiveCodeBench.
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vs. FlowBalance [5]: privileged context and optimization target. FlowBalance permits reference solutions or task feedback as training context and fits a normalized complete-response distribution through trajectory balance. RLSR constructs hindsight from its own verified search outcomes, reshapes original-attempt advantages, and explicitly trains recovery through its reflection objective. Our reproduction uses reference-solution context for FlowBalance and self-generated hindsight for RLSR; the comparison below states this supervision difference and reports results under the shared maximum trajectory budget.
We additionally evaluated FlowBalance on our training split with the same Qwen3-4B backbone, maximum trajectory budget, and evaluation metrics:
| Method | Training supervision in this comparison | AIME 2024 (avg@16) | AIME 2025 (avg@16) | MATH-500 (avg@4) | LiveCodeBench (Pass@1) |
|---|---|---|---|---|---|
| GRPO | verifier outcomes | 63.33 | 60.83 | 95.50 | 47.81 |
| RLSD | verifier outcomes and self-distillation | 66.46 | 62.44 | 94.40 | 48.52 |
| FlowBalance [5] | reference-solution context and verifier outcomes | 71.25 | 63.33 | 95.20 | 48.90 |
| RLSR (Ours) | self-generated hindsight and verifier outcomes | 74.00 | 65.09 | 95.70 | 50.30 |
Without reference-solution context, RLSR has the highest reported mean on all four benchmarks in this comparison, exceeding FlowBalance by 2.75, 1.76, 0.50, and 1.40 percentage points, respectively. These results support the effectiveness of supervision generated through RLSR's grouped search and reflection. The comparison matches maximum trajectory budgets; equal total training compute has not been established for FlowBalance.
Response to Weakness 4: Novelty justification (2/2)
The overall algorithmic distinctions are summarized below:
| Method | Training-time guidance | Additional guidance source | Credit / optimization target | Policy internalization | Correction training |
|---|---|---|---|---|---|
| SCoRe [1] | self-generated attempts and verifier rewards | own attempts | outcome and progress rewards | both attempts in Stage II | explicit; reported two-attempt curriculum |
| RLSD [2] | same-model privileged teacher | training context | token-level magnitude adjustment | verifier-directed policy updates | no explicit retry objective |
| AgentOPSD [3] | skill-conditioned teacher | retrieved SkillBank skills | recursive turn-level reweighting | agent policy updates | interactive-turn training |
| SEED [4] | evolving on-policy hindsight | external annotations for initial skill-SFT; own policy during RL | outcome RL and gated token-level distillation | ordinary agent policy | interactive-turn training |
| FlowBalance [5] | privileged hindsight and verifier rewards | reference solution or task feedback | complete-response trajectory balance | first-attempt response distribution | no explicit retry objective |
| RLSR (Ours) | verified-group hindsight and verifier rewards | own grouped search | reasoning-unit reshaping and retry returns | direct track (Table 1) | reflection track (Table 3) |
We will incorporate this taxonomy, the FlowBalance comparison and reproduction details, and the expanded discussion of SCoRe and the other related methods into the revised manuscript.
References
[1] A. Kumar et al. Training Language Models to Self-Correct via Reinforcement Learning. arXiv:2409.12917, 2024. https://arxiv.org/abs/2409.12917
[2] C. Yang et al. Self-Distilled RLVR. arXiv:2604.03128, 2026. https://arxiv.org/abs/2604.03128
[3] Z.-H. Wang et al. AgentOPSD: Recursive Self-Distillation for Agentic Reinforcement Learning. arXiv:2608.05987, 2026. https://arxiv.org/abs/2608.05987
[4] J. Wu et al. SEED: Self-Evolving On-Policy Distillation for Agentic Reinforcement Learning. arXiv:2607.14777, 2026. https://arxiv.org/abs/2607.14777
[5] Z. Huang et al. FlowBalance: Verifier-Grounded Self-Improvement from On-Policy Reasoning Experience. arXiv:2609.03241, 2026. https://arxiv.org/abs/2609.03241
Response to Weakness 1 and Weakness 2
We sincerely thank the reviewer for raising concerns about the zero direct-track signal for all-failed Marginal-ZPD groups, the limits of binary recovery credit and hindsight validation, the ZPD criterion and ablations, novelty relative to prior methods, and the strength and efficiency evidence. We address each below; shared definitions and results appear in our Common Response, C1–C5.
Response to W1: Nonzero direct-track signal for Marginal-ZPD groups
The reviewer is correct that the prompt-level GRPO estimator printed in the submission would give zero advantage to an all-failed initial group. We acknowledge that the manuscript omitted a substantive implementation detail: in practice, the direct-track baseline is computed from raw initial-attempt rewards across the admitted mini-batch, not within each prompt group. For a Marginal-ZPD attempt, this gives Aseq=−Rˉbatch/(σbatch+ϵ0)<0 whenever the admitted batch contains a positive initial reward. Common Response C3 specifies the estimator.
The successful retry supplies the reference for generating hindsight, which is then used to rescore the original failed attempt. On that attempt, a positive standardized likelihood contrast zk attenuates the step's negative advantage, while a negative zk amplifies it, within the prescribed bounds. Thus, reflection affects the relative penalties applied to the original attempt even though every initial rollout in its prompt group failed. This is the reflection-to-direct learning path implemented by RLSR.
If all initial rewards in the entire admitted batch are zero, the implementation skips the direct-track update and trains only the reflection track (which is never encountered in our experiments, see Figure 3). We will correct Section 2.4 and Algorithm 1 to specify both the batch-level estimator and this edge case.
Response to W2: Reflection credit and unaccounted win rate estimation
We agree that the estimator needs an explicit definition and that a binary outcome cannot distinguish logical progress among failed retries. In the implementation, wi,n=R(τn(i))∈{0,1} is the verifier outcome of the single retry generated at turn n. It requires no additional success-rate estimation rollouts. Eq. (3) uses the fixed initial prior plus this current outcome; with early stopping on success, ΔBn is zero on failures and positive at recovery. Failures are penalized not by a negative belief gain (as ΔBn=0), but uniformly via the step efficiency penalty −ηstep to discourage verbose looping. Common Response C1 gives the exact definition.
The term therefore supplies a prior-dependent recovery bonus. Eq. (6) propagates that reward to preceding retry turns through discounted returns, and Eq. (7) normalizes returns among active branches at the same retry depth. We will revise Section 2.3 to distinguish this recovery-based credit from direct evaluation of intermediate reasoning and to describe depth alignment without implying identical failure histories.
Its empirical contribution is isolated in Common Response C2: setting αprog=0 retains both tracks, the discounted return, peer normalization, and the step penalty. Removing the term lowers AIME 2024/2025 by 1.35/1.20 percentage points at 1.7B and 3.70/1.79 points at 4B. These results support the contribution of the recovery bonus within the full training objective; we will add them to the ablation section.