- Rating
- 3(+1)
- Confidence
- 3
- Informativeness
- 2
- Presentation
- 2
- Soundness
- 3(+1)
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Paper summary
The paper introduces a benchmark for industrial inspection agents that integrates multimodal evidence acquisition, robot tool use, and operational decisions. It defines and evaluates five agent abilities and reveals substantial gaps between terminal decision accuracy and evidence-grounded success.
Critical strengths
- The proposed environment and benchmark are a meaningful integration of agent-based physical evidence acquisition and downstream operational decision-making in a real-world application field.
- The scenario generation is well-controlled, and the design of the trace-level evaluation is rational for diagnosing agent failures beyond terminal accuracy.
Critical weaknesses
- The paper acknowledges that evidence delivery does not establish correct reasoning, which limits how strongly the reported TDA–GSR gaps can be interpreted as evidence-grounding failures. Therefore, the bench seems to be only for an inspection application evaluation rather than a solid agent capability test.
- The agent evaluation protocol and empirical controls are insufficiently specified to fully support reproducible and discriminative model comparisons.
Questions for authors
- What is the detailed agent architecture or the harness used in the evaluation? Does the benchmark environment support different or even customized agent harnesses?
- How often do successful episodes contain explicit references to the relevant observations? For temporal grounding, how does the metric distinguish actual reliance on outdated observations from legitimate decisions not to re-observe under resource constraints?
- Could the authors distinguish constructed, attempted, successfully executed, excluded, and scored episodes for each model and capability?
5 comments
Response to Reviewer Mgp9 -2/3
W1 (Part 2). Capability-Decomposed Evaluation & Empirical Longitudinal Grounding
[W1 (Continued)] "...Therefore, the bench seems to be only for an inspection application evaluation rather than a solid agent capability test."
More broadly, InspectionBench is designed as a capability-decomposed benchmark for the physical-to-operational agent lifecycle rather than a narrow application test or generic tool-calling benchmark. It complements τ/τ²-bench (tool-agent-user policy adherence) and AssetOpsBench (enterprise asset workflows) by isolating the core operational bottleneck motivated in Sec. 1 (p. 1): industrial telemetry generates far more anomaly alerts than operators can dispatch crews for (with field deployments such as ANYbotics reporting >70% false-positive alarms when unverified physically). An IoT-only agent (DIGITAL_ONLY) that acts without physical grounding either floods operations with false escalations or makes unverified commitments (as seen in our unsupported-commitment rates and 23.2–29.8 pp TDA–GSR gap).
Evaluating agents across our 24,601 replayed operational records and longitudinal compressor/plant failure trajectories (MetroPT-3 / FutureSim chronological replay; App. N, N.1, pp. 39–40, Figs. 14–15) empirically demonstrates why each of our five capabilities is necessary to govern downstream forecasting and intervention reliability:
- (A) Evidence Grounding & False-Alarm vs. Fault-Visibility Trade-off (App. N, Fig. 14, pp. 39, 45): Across 76 false incidents and 11 documented true failure incidents in the chronological replay, comparing alert-time telemetry (
R1e), decision-time telemetry (R1m), and robot-acquired physical inspection framing (R2r) against oracle-survey (R2o) and rule baselines (R3) makes the operational trade-off explicit: physical verification suppresses unnecessary escalations on false telemetry alarms while preserving high fault visibility on true incidents (Fig. 14, p. 45). - (B) Active Acquisition (ADA 0.985–1.000, ASA 0.911–0.933,
TDA_post0.167–0.727; Sec. 5.1, p. 10; App. I.4, Table 21, p. 36): Recognizes when initial telemetry or acoustic evidence is ambiguous and selectively triggers complementary acquisition before a developing fault crosses failure thresholds, while exposing that post-acquisition interpretation (TDA_post, where models over-escalate in 36%–82% of adequate-evidence episodes) is the primary bottleneck. - (C) Procedural Execution (ordering up to 100% vs. coverage down to 0.12; Sec. 5.2, p. 10; App. I.5, p. 33): Ensures multi-step diagnostic and safety protocols are substantively completed rather than superficially ordered before clearing an asset back to service.
- (D) Relational Physical Grounding (37.2 pp gap between terminal accuracy and exact physical-constraint recovery; Sec. 5.2, Fig. 7, p. 10; App. M, Fig. 13, p. 38): Certifies via a MuJoCo-backed admissibility verifier that the agent identifies the governing physical constraint (reach, clearance, joint/collision, stability, energy) or active enterprise work-order lockout (App. I.2, Table 19, p. 34) rather than guessing the right action for the wrong physical reason.
- (E) Temporal Grounding & Chronological Failure-Forecast Evolution (App. B.5, Table 8, p. 24; App. N.1, Fig. 15, pp. 40, 45): Directly governs longitudinal monitoring across chronological streams. In our February 2020
MetroPT-3chronological replay across five 24-hour windows (App. N.1, Fig. 15, p. 45), comparing IoT-only (Condition A) against budgeted physical gauge requests (Condition C, 115 valid hourly 6-hour failure forecasts per arm) shows that once the daily observation budget is spent, forecast probabilities drift upward across all windows (Spearman ρ > 0 in all 10 window-condition pairs, reaching ≥ 0.9 in 29/115 forecasts underCondition Cvs. 0/115 underCondition Adespite zero true failures). This directly motivates Capability E's resource-aware temporal validity evaluation (TVR^RA= 97.4%–100% for four models vs. 49.6% for Qwen, which commits on stale readings in 62.4% of budget-exhausted visits; Table 8, p. 24).
Response to Reviewer Mgp9 -3/3
W2, Q1 and Q3. Reproducibility, Reference Harness, Empirical Controls and Episode Accounting
W2: "The agent evaluation protocol and empirical controls are insufficiently specified..." Q1: "What is the detailed agent architecture or the harness used in the evaluation? Does the benchmark environment support different or even customized agent harnesses?" Q3: "Could the authors distinguish constructed, attempted, successfully executed, excluded, and scored episodes for each model and capability?"
We expanded Sec. 4–5 (pp. 7–9), App. A–B (pp. 17–24), App. K–L (pp. 35–37; Tables 30–34, pp. 42–43), and the Reproducibility Statement (p. 11) to specify all protocol details, controls, and step-by-step reproduction commands (REPRODUCE.md).
Q1. Harness and agent architecture (App. A, Fig. 8)
- Reference harness: Fig. 8 (p. 17) illustrates our deterministic two-call loop. Turn 1 provides asset context and regime-masked tool names (25
FULL, 23PHYSICAL_ONLY, 22DIGITAL_ONLY), executing the first 8 requested calls auto-bound toasset_id. Turn 2 returns structured JSON observation records (status,observation_id,observation_hash,modality,payload,observed_at) for the terminal verdict and citations. Verbatim prompts, a full episode transcript, and frozen settings are in Listings 1–3 (pp. 18–19) and Table 30 (p. 42). - Custom harnesses: We expose 67 tools across 7 FastMCP servers with full JSON schemas (App. A.5, p. 19) registered in AssetOpsBench's registry so any MCP-compatible SDK or multi-turn runner can attach over stdio. Because exposing full schemas in a 1-round, 8-call loop shifts agent behaviour (App. A.7, Table 6, p. 20), custom-harness runs should be compared with each other rather than Fig. 5.
- Call-lifecycle audit (Table 5, p. 20): Auditing all 14,440 traced episodes confirms 0 calls failed on arguments/syntax and 0 of 26,612 executed gold-determining calls failed.
W2. Capability scoring and empirical controls (App. B, K.5–K.7, L.1)
- Deterministic scoring: Every metric across Capabilities A–E is a pure Python function of the response and hash-chained trace with no LLM judge (missing/invalid outputs score 0; formal definitions in App. B.1–B.5, pp. 21–24).
- Pre-run empirical controls & reproduction: In App. B.6, K.5, and L.1 (pp. 24, 35–37), we document our fixed reference policies, matched regimes holding world/gold fixed, paired world-cluster bootstrap CIs (B = 10,000, Holm-corrected), and pre-registered 237-episode repeat audit (Table 34, p. 43), ranking models only where paired CIs exclude zero. To easily verify all results, we invite the reviewer to follow our 5-step walkthrough in App. K.6 (p. 36) and
REPRODUCE.mdin the anonymous repo, which provides direct scripts (compare_runs.py) for API-free CPU rescoring, episode regeneration, and full re-runs (compute/cost in Table 32, p. 43).
Q3. Episode accounting (App. K.2, Table 31, p. 42)
- Episode breakdown: Table 31 (p. 42) tracks every episode per capability and model: of 4,120 constructed canonical episodes, a pre-run script excluded 49 (observationally identical seeds in A/E or unreachable route gold in D-enterprise), leaving 4,071 eligible episodes attempted and scored for every model with 0 remaining infrastructure failures (invalid/missing outputs remain in the denominator and score 0).
Q2 (Part 2). Temporal Grounding under Resource Constraints
Q2 (Part 2): "For temporal grounding, how does the metric distinguish actual reliance on outdated observations from legitimate decisions not to re-observe under resource constraints?"
Thank you, this question exposed a real gap, which we audited directly from our frozen traces without re-running models (Sec. 5.3, p. 10; App. B.5, Table 8, pp. 23–24; App. F.5, Table 15, p. 29). Because physical reads draw on a sequence budget β = n − 1 and are refused once spent, original TVR did not separate stale reliance from forced inability to re-observe (we also corrected App. F.5 on SEQ-06001 ep. 2). Classifying all 4,690 repeated episodes (469 sequences/model; Table 8, p. 24) separates fresh reads (1,949), budget-feasible stale reliance (0 of 542), budget-exhausted safe abstentions (ESCALATE/ABORT, 2,193), and budget-exhausted commitments (483, concentrated in Qwen at 62.4% [472/757] and DeepSeek at 2.4% [11/463], with 465/483 rationales explicitly citing earlier visits). We therefore added Resource-Aware TVR (TVR^RA), which exempts budget-exhausted abstentions while penalizing ungrounded COMMITs, shifting repeated-episode TVR from 41.7–50.6% (19.2% Qwen) to 97.4–100.0% for four models versus 49.6% for Qwen (Table 8, p. 24).
If these answers resolve your concerns, we would be grateful if you could reflect them in your assessment.
Response to Reviewer Mgp9 -1/3
Thank you for your constructive review. Please find our point-by-point response across three comments below.
W1 (Part 1) & Q2 (Part 1). Interpreting GSR, Decomposing the TDA–GSR Gap, and Explicit Observation References
We agree that successful evidence delivery does not by itself demonstrate that an agent used the delivered evidence correctly. We clarified the interpretation of GSR and
Δ_TDA-GSRin Sec. 4 (p. 8) and Sec. 5.1 (pp. 9–10): GSR is a trace-verifiable minimum condition combining terminal correctness with successful delivery and provenance of the required physical evidence, rather than a direct measure of internal reasoning. WhileGSR = 1is a necessary floor,GSR = 0whenTDA = 1certifies that a correct action was taken without receiving the required physical observation making the 23.2–29.8 pp TDA–GSR gaps across four of five models (Fig. 6, p. 10) a conservative lower bound on ungrounded commitments.Alongside GSR, we report four complementary evaluations (Sec. 3.2, p. 6; Sec. 5.1, pp. 9–10; App. B.1, I.7–I.8, pp. 21–22, 34, 38–40):
A_I, IJA & Strict GSR, App. I.7, Tables 23–24, pp. 38–39): When physical readings are withheld (DIGITAL_ONLY, 255COMMIT-gold worlds/model), 47.1% of DeepSeek V4 Pro and 32.5% of Qwen3.5 decisions are unsupported commitments, whereas GPT-6-Astra (100%) and Claude Opus 5.5 (97.6%) choose justifiedESCALATE. Pairing this with each model's matched-worldΔCOMMITrate (FULLminusDIGITAL_ONLY: +0.36 to +0.73 for four models vs. +0.02 [−0.02, +0.05] for DeepSeek) separates evidence-dependent caution from default escalation.P(ESCALATE)rises by Δ = +0.43 to +0.90 (exact McNemar p ≤ 3 × 10⁻⁸ in every cell; only 1 reverse flip in 921 pairs).