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Paper summary
This paper introduces EvidBind-Bench, a benchmark designed to evaluate video-based, tool-using agents on their ability to make "evidence-based decisions" within hour-long video scenarios. The benchmark encompasses 3,000 tasks spanning 13 domains and five decision structures. The authors propose a "design-binding" workflow and a perception-dependency repair mechanism for task construction and validation, and evaluate ReAct and multi-agent frameworks using a variety of open-weight and API-based models.
Critical strengths
- Addresses a genuine bottleneck in long-video agent evaluation. The paper identifies an important gap in existing long-video benchmarks: successful tool execution does not necessarily imply that an action is properly supported by video evidence. The example of a customer returning and replacing a milk carton illustrates this issue well. Observing only the checkout scene may lead to an incorrect product identification if the agent fails to track the relevant object and state transitions over time. The distinction between executability and evidence support is well motivated and conceptually valuable.
- Provides a clear task formulation. The paper separates the task objective, operational constraints, required decisions, and dependencies among decisions. It also introduces a principled notion of pre-action evidence support: an action should be justified by publicly accessible evidence obtained before the action is taken, rather than by information observed only later or by hidden annotations. This is a coherent formulation of an important requirement for reliable long-video agents.
- Introduces a sizable and structurally diverse benchmark. EvidBind-Bench contains 3,000 tasks spanning 13 domains and five representative decision structures, including sequential progression, conditional branching, multi-hop dependencies, joint constraints, and plan-execution audits. The construction effort appears substantial. The paper also reports an independent human audit of 390 sampled tasks, with an estimated overall validity rate of 96.4%, which is encouraging.
- Reveals a substantial gap between current agents and human performance. The experiments evaluate Qwen, DeepSeek, and LFM models. Under the reported setup, the best multi-agent configuration achieves 17.73% success, compared with 11.23% for the corresponding ReAct baseline and 91.73% for human participants. These results suggest that the benchmark is challenging and may provide useful diagnostic signal for long-context, temporally grounded agent behavior.
Critical weaknesses
- Important reporting and reproducibility details are missing. Several appendix sections contain unresolved placeholders, including “–” and “Appendix ??”. These missing fields concern domain boundaries, task-selection rules, concrete repair examples, dependency-propagation outcomes, and implementation details. The paper also does not disclose the models, prompts, or configurations used for task generation and repair. For a benchmark paper, these details are central to reproducibility and to assessing dataset validity.
- There is a mismatch between the central claim and the evaluation metric. The paper is framed around evaluating evidence-grounded decisions, but the main metric does not directly evaluate whether an agent retrieves or uses the required video evidence. As stated in Section 3.3, the external scorer accepts any trajectory satisfying the final goal and execution constraints, while success rate measures task completion rather than evidence use or failure causes. Therefore, an agent may receive full credit if it reaches the correct final state through guessing, brute-force exploration, prior knowledge, or other shortcuts without retrieving the relevant video evidence. The evidence-binding mechanism is used to validate task construction, but it is not used to determine whether an evaluated agent's execution is actually evidence-grounded. The paper should introduce trajectory-level evidence metrics or substantially narrow its claims.
- The reported cost reduction is confounded by scale effects. Section 4.5 and Table 4 report a 72.86% reduction in combined cost per estimated valid task. However, the baseline produces 300 tasks, whereas the proposed binding-guided procedure produces 3,000 tasks. The paper acknowledges that the original goal pools are not documented as corresponding and that the comparison is conducted at unequal output scales. At the larger scale, shared video processing, initial screening, and reusable fact verification can be amortized over many more tasks. Thus, the reported reduction may reflect scale-related amortization rather than the causal benefit of the proposed binding and dependency-aware repair mechanism. A convincing comparison should use the same pre-specified task pool, matched budgets, comparable reviewer rules, and equal-scale or scale-controlled conditions.
- Shortcut risk weakens the claim of long-video temporal reasoning. Among 200 pre-specified cross-temporal tasks, 19 tasks (9.5%) could be solved through a short video window or without viewing the video at all. This raises concern that some tasks may not genuinely require long-range temporal integration. Since the main metric evaluates only final task completion, agents may exploit such shortcuts while still receiving full credit. The paper should provide stronger evidence that its tasks require the intended long-video evidence, for example through temporal-window ablations, video-removal tests, time-order perturbations, and analyses of alternative solution paths.
- The contribution is not sufficiently differentiated from related benchmarks. The paper overlaps substantially with recent work on long-video, video-grounded, and tool-using agents, including VideoWebArena, Ego2Web, EgoBench, VideoGAIA, and TaskCraft. The proposed decision-level evidence binding may be a useful distinction, but the paper does not provide a sufficiently direct comparison or controlled ablation demonstrating that this mechanism yields benefits beyond existing task-construction and validation pipelines.
Questions for authors
- Missing implementation details and placeholders. Please explain why several appendix sections contain unresolved placeholders, such as “–” and “Appendix ??”, including sections related to domain boundaries, decision rules, and repair examples. Which LLMs or multimodal models were used for task generation and repair? Why are the prompt templates, model configurations, and key implementation details not provided?
- Trajectory-level evidence evaluation. The paper introduces a structured representation that links each required decision to supporting evidence, entity correspondence, temporal scope, and action conditions. Why is this information not used to evaluate whether an agent actually retrieves and uses the required evidence during execution? Could the authors report trajectory-level metrics, such as evidence retrieval recall, evidence precision, temporal grounding accuracy, or decision-level support accuracy, in addition to end-to-end task success rate?
- Controlled cost comparison. Could the authors compare the proposed binding-guided repair method with full per-task review at the same scale, for example using 300 tasks in both conditions or 1,000 tasks in both conditions? This would help separate the benefit of the proposed method from the amortization effect caused by sharing preprocessing and review costs across a much larger number of tasks.
- Mitigating shortcut exploitation. Given that 9.5% of tested cross-time tasks can be solved via short clips or no video at all, do the authors have a systematic filtering mechanism to purge non-temporal shortcuts from the benchmark? How do evaluated agents perform under blind/no-video control settings?
8 comments
2. Response to Weakness 2 and Question 2
Summary
We report task success and Joint-SR (success with every required decision supported before action), calibrate evidence scoring, and test content dependence through matched masking.
(1) Sampling and scoring
The 300-task diagnostic sample draws visual obligations from 3,000 tasks: 23/domain plus one by a predetermined rule, across 30 videos selected before solving without filtering on clarity, shortcuts, or scores. Full-benchmark SR remains 11.23%/17.73% for ReAct/five-role; diagnostic SR is ReAct 118/900 (13.11%), five-role 154/900 (17.11%) over three seeds. These denominators are distinct and establish no equivalence. Q2 and Q4 share backbone, caps, seeds, and Joint definition, but use separate episodes/observations; Q4 imports no Q2 trajectories. Matching seeds do not identify matching episodes.
Rules verify source versions, delivery, action order, and receipts. Two reviewers independent of construction/annotation judge relevance, completeness, and parameter support, with third-rater adjudication, blind to model/condition, final state, and SR. Unlisted evidence receives the same source/entity/time/sufficiency checks before uniform rescoring. Role summaries need sufficient facts and traceable receipts acquired/delivered before action; unsupported conclusions or undelivered links fail.
Calibration uses 20 videos, ten held out, with balanced SR-pass/fail strata hidden from reviewers. Per-condition samples are 150 relevance frames (75/stratum), 180 complete-evidence visual decisions (90/stratum), and 240 parameter-support decisions (120/stratum). Pooled agreement across four conditions is, respectively, 586/600 = 97.67% (κ = 0.945), 698/720 = 96.94% (κ = 0.935), and 934/960 = 97.29% (κ = 0.932). The 960 include 720 visual/240 nonvisual decisions; overlaps are not independent. Of the 26 parameter-support disagreements, 14 involve alternative evidence (8), provenance (4), or time boundaries (2). Revised held-out agreement is 470/480 = 97.92% (four false accepts/six rejects), with 90 visual/30 nonvisual decisions per condition.
The further 120 held-out trajectories include 30/condition, half SR-passing. Blinded support adjudication AND frozen SR forms Joint; 60 SR failures are automatic negatives. Among 60 SR successes, supported cases yield 39 accepts/one reject (40); unsupported cases two accepts/18 rejects (20); totals are 41/19. Agreement is 57/60 = 95.00%, versus 117/120 = 97.50% including automatic negatives. False acceptance is 2/20 = 10.00% (Wilson 95% interval 2.79–30.10%); false rejection 1/40 = 2.50%; unsupported among accepted is 2/41 = 4.88%. All results use one final version untuned on held-out checks; this pooled sample cannot establish condition-specific errors.
(2) Evidence coverage and experimental settings
Confirmed relevant positions cover 2.15% of the video grid, not exhaustive density; unannotated positions stay unknown. All accessed frames undergo relevance/boundary/alternative-evidence review, reusable only for the same task/version/location. The 128,342 within-run-deduplicated accesses are not independent judgments.
QWEN3.8-VL 27B uses seeds 17/29/43: 300 × three = 900 runs/condition; decision/vision-ranking temperatures 0.2/0.1, top_p 1.0, thinking off. Each run’s roles jointly share 180,000 input/output tokens, 48 model requests, 64 tool calls, 96 visual-frame processing events, and 900 seconds, including auxiliary calls/retries. Private-binding position hints are oracle assistance; charging them does not remove their information advantage.
Visual/total obligation denominators are fixed at 3,108/4,908 per condition, retaining unvisited/unfinished/exhausted cases. Retrieval needs a complete legal pre-action evidence combination; support also checks chosen parameters. Localization scores model-submitted pre-action intervals, not request windows: one-to-one matching to every interval of one legal combination at IoU ≥ 0.5; one broad interval cannot match separated events, and missing predictions fail. Single frames count only for registered static facts within valid intervals, with half-step boundary tolerance and correct entity mapping, never event intervals. Table 1. Trajectory evidence metrics in percent
| Condition | Complete retrieval | Frame precision | Localization | Visual support | All-obligation support |
|---|---|---|---|---|---|
| ReAct | 45.79 | 22.07 | 37.84 | 42.41 | 57.60 |
| Five-role | 53.80 | 28.97 | 46.91 | 49.20 | 63.81 |
| ReAct + oracle | 64.96 | 36.90 | 58.78 | 59.65 | 71.09 |
| Five-role + oracle | 72.23 | 44.12 | 67.60 | 68.73 | 78.14 |
For sensitivity, let S and J denote SR and scored Joint success counts. Assuming common sensitivity a = 39/40 and false acceptance b = 2/20, supported successes are (J − bS)/(a − b):
Table 2. Task success, pre-action support, and scoring sensitivity
| Condition | SR | Joint-SR | Joint-SR 95% CI (%) | Joint under shared errors (%) |
|---|---|---|---|---|
| ReAct | 118/900, 13.11% | 68/900, 7.56% | [4.00, 11.89] | 7.14% |
| Five-role | 154/900, 17.11% | 99/900, 11.00% | [6.11, 16.78] | 10.62% |
| ReAct + oracle | 183/900, 20.33% | 128/900, 14.22% | [8.78, 20.44] | 13.93% |
| Five-role + oracle | 254/900, 28.22% | 183/900, 20.33% | [15.00, 26.56] | 20.01% |
Intervals use 2,000 video-cluster bootstrap draws preserving task/seed dependence, excluding scoring uncertainty. Of 154 five-role successes, 99 score supported and 55 unsupported. The five-role–ReAct gap is 3.44 pp as scored, 3.48 under shared errors; this neither replaces counts nor proves robustness to condition-specific error. SR masking results (154→31 versus 152) independently test content dependence, conditional on SR-checker validity, not internal reasoning.
(3) Regenerating actions after frame removal
Each arm removes 6,976 frames across 900 unassisted five-role runs, matched per run, with fixed acquisition/no replacement. Controls are confirmed irrelevant outside all sufficient combinations. From before the first affected observation, regenerate judgments, role messages, memory, parameters, actions, and tool returns; reuse no removed evidence, summaries, IDs, or receipts.
Table 3. Fixed-schedule content intervention
| Condition | SR | Joint-SR | SR change, pp [95% CI] |
|---|---|---|---|
| Full observations | 154/900, 17.11% | 99/900, 11.00% | — |
| Selected key evidence masked | 31/900, 3.44% | 2/900, 0.22% | −13.67 [−18.56, −9.55] |
| Matched irrelevant frames masked | 152/900, 16.89% | 97/900, 10.78% | −0.22 [−0.89, 0.44] |
Key masking yields 128 success→failure/five failure→success, with 26 stable successes/741 failures. Irrelevant masking yields five success→failure and three failure→success transitions, leaving 152 successes. These exhaust runs; intervals cluster by video. SR tests fixed-schedule content dependence; Joint additionally enforces support. Neither establishes individual internal reliance.
Author Response to Reviewer NpeF
Thank you for recognizing evidence-supported decisions. We address your concerns below and will revise the paper and appendices together after discussion. Attachment A provides construction prompts, frames, reference traces, and version-bound reviews; B records a separate solving episode with the same abstract goal but a different frozen instance and trajectory. We welcome feedback and would appreciate reconsideration if these responses resolve your concerns.
1. Response to Weakness 1 and Question 1
Summary
We provide the construction recipe, domain/audit criteria, and a complete supermarket record from design through binding repair, review, and reference reruns.
(1) Construction and implementation
We apologize for the unfilled entries and unresolved “Appendix ??” references. Incomplete implementation reporting and cross-reference checks made the procedures harder to verify. The two attachments provide configurations and process records. After discussion, we will complete the reporting and check cross-references in the paper and appendix. In Attachment A, Designer API_1 receives the complete Retail construction/review exemplar, public goal, five catalogue rows, and tool contracts; it freezes goals, constraints, decisions, and dependencies before source-frame decoding, without target time, pixels, or answer. Schema-specified obligations/edges constrain generation. Bindings add sources, entity correspondence, applicable time, and action conditions; repair receives old/new records and gaps without weakening requirements or scope. Source/interface/precondition/budget checks precede selection; uncertain effects require full review and fresh-state replay. Support requires a nonempty interpretation set and a choice valid throughout; conflicts/decision-changing ambiguity remain unresolved. Replay and human approval are separate.
Qwen3.8-27B uses temperature 0.1 for all construction roles, top p 1.0, and thinking off. Per-call seeds include Designer API_001 = 7315 and visual API_006 = 7320; complete parameters are recorded. All 38 requests, including earlier attempts/post-H1 revision, use 0.1: the earlier 0.2/seed-17 summary was incorrect, not version drift. Construction, Q2 solving, and Q3 cost budgets/settings are separate.
(2) Worked example and audit scope
The task identifies the bag unfolded later near checkout, orders one matching variant, and links an awaiting-arrival check to the new order while preserving existing records. Video supplies identity, instructions quantity, and execution the order ID; five catalogue rows are authored comparisons, not observed products.
The 24 coarse samples provide no observation meeting the supplied 1995s anchor’s time-applicability condition; API_4 admits no binding and no order is attempted. API_5 proposes six nearby times for fresh VLM API_6 observations. API_7 returns three bindings, deduplicated by exact object and ranked lexicographically by validation failures, declared extra accesses, and proposal index. The selected receipt binds the 1995s observation (“Yonghui Life”, dark green) to ITEM_F1514293DB09 via an explicit semantic adapter. Goal, anchor, and candidate universe stay fixed; reacquisition and revalidation address the unmet support check.
Two isolated Qwen references execute catalogue → fresh video/VLM inspection → order permission → order → read order receipt → check permission → linked check → finish. Operators receive bindings, testing reference executability rather than blind performance. The opaque purchase handle leads to the new order ID through read order receipt. None of the three references, including the later revision, calls list records; state reads are audit hooks. Runtime permissions differ from review approval.
A’s five-candidate construction_v4 uses 25 main calls/137,623 tokens and 10 post-H1 calls/29,877 tokens; its 38-request registry includes three across two failed runs. B’s four-candidate seed_511 v5 uses 19 requests/107,918 tokens/five tool calls. These are distinct frozen instances, not paired performance runs.
On 14 November 2026 at 15:09 +08:00, H1 passes facts, tools, and task/repair, requesting distractor ITEM_26857A389CAB change from unknown color to red—an authored catalogue edit, not video fact. The 10-call rebinding/fresh-observation/reference rerun passes revised DB/trajectory review at 15:39. Approval/reuse is version-bound and excludes B. H1 confirms “Yonghui Life” and green, not separately dark green; B’s audit reads are not agent actions.
Domains follow end states: buying/shelving/stock allocation; food preparation/use/storage; object assembly/restoration. Unknowns stay unknown. All five structural labels remain, but only primary multi-hop/plan-audit defines the complex subset. The separate original audit randomly samples 390/3,000 without replacement/quotas: 376/390 valid, including 145/156 complex. Independent double review, adjudication, and unresolved-case failure apply.