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Under review as a conference paper at ICLR 2027

Learning to Scale at Test Time: RL from LLM Feedback Loops

Abstract

Test-time scaling improves large language model reasoning by allowing models to explore, revise, and aggregate multiple attempts. Reinforcement learning (RL) offers a way to develop these capabilities, but training on extensive interaction trajectories can be costly, and the value of different training data remains poorly understood. In this work, we investigate how to select useful RL contexts and learn from offline solution attempts and feedback. We construct a dataset of 200K offline trajectories by iteratively generating solutions and feedback for 6K mathematics problems. Through extensive post-training experiments on this dataset, we identify important factors such as solution diversity, loop count, and surprisingly irrelevant factors such as orchestration topology. To put these findings into practice, we select trajectories from the latest revision round that satisfy accuracy and diversity constraints for each problem. Using these selected data, we train Qwen3.5-4B without additional supervised fine-tuning, achieving 82.5% accuracy on IMO-AnswerBench with test-time scaling, surpassing DeepSeek-Math-V2 (75.8%) and Gemini Deep Think (IMO Gold, 80.0%). Our trained Qwen3-4B model also matches QED-Nano's accuracy with approximately half the inference compute.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Large Language Model, Reinforcement Learning

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_gMn3OpenReview ↗
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Paper summary

This paper incorporates loop-based refinement into reinforcement learning. Specifically, the authors provide the model being trained with incorrect responses and corresponding failure analyses generated by a high-performing model. They also use failure diversity as a criterion for selecting training data. In my view, the core idea is interesting. However, the practical relevance of the proposed method remains unclear, and the overall framework appears overly complex and computationally expensive.

Critical strengths
  1. The paper is well written and easy to follow.
  2. The paper presents an interesting perspective by combining loop-based refinement with RL training.
Critical weaknesses
  1. The proposed method incurs substantial computational costs and relies on an external high-performing model to generate feedback. It remains unclear whether this approach offers advantages over directly distilling knowledge from that model.
  2. The comparison between LoopRL and the other models in Figure 1 appears unfair, as the other models do not have access to previous trajectories and feedback.
Questions for authors
  1. How can prompts for which all sampled solutions fail benefit from GRPO training? If all solutions receive the same reward, their advantages should be zero, resulting in no policy-gradient learning signal.
  2. Feedback from a stronger model may reveal the correct solution or the reasoning path leading to it. How do the authors rule out solution leakage as the source of the observed gains? More broadly, which contributes more to LoopRL’s performance: the previous trajectory or the feedback?
  3. What does the reported value of 82.5% represent? The main text describes it as pass@8 at loop 11, whereas line 697 attributes it to loop 0. Could the authors clarify this discrepancy?
  4. Why does feedback from later loops lead to better performance? Do the authors have empirical observations or analyses that explain this finding?
  5. What real-world application scenarios do the authors envision for the proposed method?
1 comment
AuthorsOpenReview ↗

Response to Reviewer gMn3

Thank you for the comments. The stronger teacher, Qwen3-235B-A22B, only writes feedback during offline data collection. During RL, the policy generates a fresh solution and earns a reward for its final answer. At test time, the evaluated model writes its own feedback. Moreover, we trained Qwen3-4B on the same LoopRL’s selected contexts after removing their feedback. At inference time, this variant directly revises or aggregates its previous solutions, whereas standard LoopRL also has the evaluated model generate feedback. The two models reach 79.33% and 79.32% mean accuracy. These results indicate that context selection is the main source of LoopRL’s gains. Appendix B.8 reports all scores alongside the solution-only training curves.

W1 / Q2: The stronger teacher is used only for offline feedback collection. At inference, the evaluated 4B model produces both solutions and feedback itself, where feedback receives only the question and the model's solution. If the model derives the correct answer in its own feedback, that is part of its inference, not information supplied by a teacher. LoopRL studies RL from interaction states: the previous attempt and feedback condition a fresh solution that must earn a verified reward. We don’t study SFT, and thus neither stored solution nor feedback is a supervised response target.

Moreover, we add an experiment for comparing solution-only and solution-plus-feedback training (Appendix B.8). Both variants train on the same selected questions and stored solutions. Standard LoopRL (solution-plus-feedback) also conditions on stored feedback, whose tokens are excluded from the policy loss. At inference it generates its own feedback, while the solution-only model revises or aggregates its previous solution directly. Standard LoopRL scores higher on AIME 2026 and IMO-Answerbench, and the solution-only variant scores higher on both HMMT benchmarks. With selected contexts, solution-only reaches 79.33% versus 79.32% with feedback (Table 5). Figure 4 additionally demonstrates the selection benefit on the same questions. These results indicate that context selection is the main source of LoopRL’s gains; explicit feedback provides no gain in mean accuracy.

W2: We report question-only loop-0 accuracy: 63.8% for LoopRL-Qwen3-4B and 69.0% for LoopRL-Qwen3.5-4B. During iterative inference, each evaluated model generates its own solutions and feedback. Figure 5 compares base and trained models under the same feedback scaffold. We additionally give QED-Nano access to previous trajectories and self-generated feedback through this same scaffold (Appendix B.9, Table 7). It reaches 76.19% at 57.85 effective PFLOPs, compared with 76.44% at 33.21 for LoopRL-Qwen3-4B and 82.50% at 42.81 for LoopRL-Qwen3.5-4B. Applying extended scaling to all larger models exceeds our inference resources.

Q1: The reviewer is correct that a fresh GRPO group with identical rewards has zero group-relative advantages. “All incorrect” describes eight offline continuations used to characterize a context. Training samples a fresh group from the current policy, which can contain both correct and incorrect solutions. Zero offline successes therefore does not imply zero training signal. Diversity distinguishes these failure states: diversity=2 contexts reach 79.8%, compared with 75.0% for diversity=1 contexts.

Q3: The headline 82.5% is LoopRL-Qwen3.5-4B's mean accuracy at inference loop 11. Appendix B.2 reports a separate result: LoopRL-Qwen3-4B's loop-0 pass@8 is also 82.5%.

Q4: Appendix B.7 already gives a possible way to explain the result that different loops lead to different RL outcomes. We compute NLL of prompts from loops 1–4 and compare it with mean prompt length. Mean prompt NLL decreases from 1.1473 at Loop-1 to 0.9855 at Loop-4, while prompt length is not monotonic. (Table 6)

Q5: Agent harnesses repeatedly propose, observe, and revise. Code generation with test failures, proof search with verifier feedback, and tool-using agents all produce reusable intermediate states. LoopRL provides a training recipe for these loops: select useful states and train short on-policy continuations, even when deployment uses repeated revision or aggregation.

In conclusion, we systematically studied which data from multi-loop reasoning trajectories are most useful for RL training, and proposed the data selection method from the experiments. Training on the selected 5.2K contexts brought a 4B model to the IMO gold medal level. The 4B model reaches 82.5% on IMO-AnswerBench, above the reported 80.0% score of Gemini Deep Think (IMO Gold) on that benchmark. We release all training code and data to enable reproduction and further study of RL on feedback loops.

Reviewer_jVx2OpenReview ↗
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Informativeness
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Paper summary

LOOPRL studies how solution traces and feedback generated offline can serve as context for reinforcement learning. The authors collect approximately 200,000 interaction records from approximately 6,000 mathematics problems and investigate the effects of sampled-answer correctness rates, answer diversity, collection rounds, and different ways of combining solutions and feedback. For each retained problem, LOOPRL selects the context from the latest collection round that satisfies the correctness and diversity criteria, then uses GRPO to optimize responses newly sampled under that context. The paper evaluates two 4B Qwen models and reports improvements with multi-round revision and multi-branch aggregation at test time.

Critical strengths
  1. Controlled comparisons support context selection,The improvements over the base models are substantial. Using the same problems and training settings, LoopRL reaches 81.4% mean accuracy across the three HMMT/AIME benchmarks at step 100, compared with 79.9% for random contexts and 78.1% for problem-only training. This supports both the use of historical contexts and the benefit of selecting them.
  2. The selected data transfer across model initializations and improve test-time scaling. Reusing the same offline data for Qwen3.5-4B yields 82.5% on IMO-AnswerBench at loop 11, compared with 77.3% for its base checkpoint. Under the authors’ evaluation, the Qwen3-4B variant also matches QED-Nano’s 76.4% at 33.21 rather than 64.64 PFLOP per problem.
Critical weaknesses

1.The loop-depth comparison does not fully control for problem composition. Section 3.3 and Appendix D.6 match subset sizes and the marginal distributions of accuracy and answer diversity, but do not specify whether the subsets contain the same problems or match the joint distribution of these statistics. The increase from 72.8% at LOOP-0 to 81.1% at LOOP-4 could therefore partly reflect differences in problem composition. Since the empirical study is the paper’s main contribution, please clarify the matching procedure and report variability for the key comparisons. 2. The contribution of feedback itself is not isolated. Section 4.2 compares problem-only training with random and selected solution–feedback contexts. These comparisons support the overall recipe, but do not isolate the benefit of feedback beyond the stored solution. A comparison of solution-only and solution-plus-feedback training, holding the selected problems, stored solutions, and training budget fixed, would clarify this contribution. 3. The evidence for several small differences underlying the main empirical conclusions remains insufficient. Selected-context training outperforms random-context training by 1.5 percentage points. In Table 1, using contexts from round 2 in both cases, training with a single solution-feedback pair and with three solution-feedback pairs achieves 71.1% and 70.5% on IMO-AnswerBench, respectively. LOOP-4 and LOOP-1+2+3 achieve 72.0% and 71.9%, respectively, but this latter comparison also changes the collection rounds. The results support the conclusion that training with a single solution-feedback pair can transfer to inference with aggregation, but they do not yet support the broader statement in the abstract that orchestration topology does not matter.

Questions for authors

Please address Critical Weaknesses and clarify the following:

  1. The evaluator in Figure 17 outputs “judgment correct,” “reveals final answer,” and a quality score. Are the two flags used to filter or rank branches, or only recorded? What fractions of selected feedback make an incorrect judgment or give away the final answer? This would clarify the information present in the training contexts.
  2. Section 4.3 describes QED-Nano’s configuration as summary-based, whereas the RSA scaffold in Appendix B of its original paper includes final candidate selection. Which configuration did you use, and does 76.4% measure average correctness across final-round candidates or the accuracy of the selected output? Please state the grading rules and which summarization, generation, and selection calls are counted in 64.64 PFLOP, so that the claimed 48.6% compute reduction can be assessed as a comparison of complete inference pipelines.
  3. On exactly the same set of questions as in Figure 4, with the training settings and number of steps held fixed, how does always using the context from the final collection round compare with the proposed selection rule?
  4. Do the groups in the round comparison use the same questions and match the joint distribution of correctness and diversity? If not, can a comparison on the same set of questions confirm that the advantage of contexts from later rounds persists?
  5. How stable are the key comparisons in Figure 4 and Table 1 across repeated training and evaluation runs? Please report variability across random seeds, as well as uncertainty estimates using questions as the unit of analysis.
1 comment
AuthorsOpenReview ↗

Response to Reviewer jVx2

Thank you for the comments. We trained Qwen3-4B on the same LoopRL’s selected contexts after removing their feedback. At inference time, this variant directly revises or aggregates its previous solutions, whereas standard LoopRL also has the evaluated model generate feedback. The two models reach 79.33% and 79.32% mean accuracy. These results indicate that context selection is the main source of LoopRL’s gains. Appendix B.8 reports all scores alongside the solution-only training curves. We also added a comparison of QED-Nano and both LoopRL models under our feedback scaffold, with loop-specific accuracy and effective PFLOPs in Appendix B.9.

W1 / Q4: Figure 3b matches the marginal distributions of accuracy and diversity, with 1,628 contexts per arm. Joint matching across depths leaves very few usable contexts, so we use marginal matching to retain a meaningful training set. Figure 4 separately holds the questions fixed: selected, random, and problem-only contexts achieve 81.4%, 79.9%, and 78.1% mean accuracy at training step 100.

W2: We add an experiment for comparing solution-only and solution-plus-feedback training (Appendix B.8). Both variants train on the same selected questions and stored solutions. Standard LoopRL (solution-plus-feedback) also conditions on stored feedback, whose tokens are excluded from the policy loss. At inference it generates its own feedback, while the solution-only model revises or aggregates its previous solution directly. Standard LoopRL scores higher on AIME 2026 and IMO-Answerbench, and the solution-only variant scores higher on both HMMT benchmarks. With selected contexts, solution-only reaches 79.33% versus 79.32% with feedback (Table 5). Figure 4 additionally demonstrates the selection benefit on the same questions. These results indicate that context selection is the main source of LoopRL’s gains; explicit feedback provides no gain in mean accuracy.

W3 / Q5: Table 1 shows that single-pair training transfers to three-pair aggregation inference: Loop-2 and Loop-2×3 achieve 71.1% and 70.5% on IMO-AnswerBench. Loop-4 and Loop-1+2+3 achieve 72.0% and 71.9%. We express the abstract's finding directly: “… training on a single solution-feedback pair transfers effectively to multi-branch aggregation at inference.” The key comparisons use one training seed. Repeated training runs have not been performed because of their substantial cost.

Q1: Both evaluator flags are hard filters, followed by ranking on feedback quality. We removed 25.72%/34.60%/26.87%/28.76%/26.64% items with incorrect judgments and 26.67%/22.69%/22.93%/21.20%/22.56% items that revealed the final answer for loop 0-4, respectively.

Q2: We ran QED-Nano’s RSA generation and aggregation stages without final candidate selection, since final candidate selection does not improve performance in our experiments. Its 76.4% is mean correctness across final-loop candidates. The 64.64 PFLOP includes summarization and generation. At the same 76.4%, LoopRL uses 33.21 PFLOP, giving the reported 48.6% reduction. All candidates use the same DeepSeek-V4-Flash-0731 final-answer-equivalence judge, without partial credit.

We additionally evaluated QED-Nano with our feedback scaffold and report all five loops in Appendix B.9, Table 7. It achieves 76.19% at 57.85 effective PFLOPs, versus 76.44% at 33.21 for LoopRL-Qwen3-4B and 82.50% at 42.81 for LoopRL-Qwen3.5-4B. These models give accuracy gains of 0.25 and 6.31 points with 42.6% and 26.0% less effective compute, respectively.

Q3: Our rule chooses the latest eligible context and falls back to an earlier loop when necessary. Figure 4 compares selected, random, and problem-only contexts on the same questions. Thanks for the comment, but we have not run the additional always-final-round comparison because of its substantial cost; the full final training run requires 1,632 H200 GPU-hours.

In conclusion, we systematically studied which data from multi-loop reasoning trajectories are most useful for RL training, and proposed the data selection method from the experiments. Training on the selected 5.2K contexts brought a 4B model to the IMO gold medal level. The 4B model reaches 82.5% on IMO-AnswerBench, above the reported 80.0% score of Gemini Deep Think (IMO Gold) on that benchmark. We release all training code and data to enable reproduction and further study of RL on feedback loops.

Reviewer_SWybOpenReview ↗
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2
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3
Informativeness
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Paper summary

This paper studies offline solution–feedback contexts for on-policy RL. Controlled ablations suggest that answer diversity identifies useful all-incorrect prompts, later-loop contexts are more useful after matching accuracy and diversity, and single-pair contexts transfer to multi-branch aggregation. LoopRL selects the latest context per problem subject to accuracy and answer-diversity constraints, then applies GRPO without additional SFT. The resulting Qwen3.5-4B reaches 82.5% on IMO-AnswerBench with test-time scaling.

Critical strengths
  1. Decoupling offline contexts from on-policy responses lets one dataset emulate many orchestration topologies without collecting new targets.

  2. Provides systematic ablations and a useful same-problem comparison against problem-only and random-context training.

  3. Demonstrates substantial gains on two 4B models, with the selected contexts transferring to a different model without regenerating data.

Critical weaknesses
  1. Gains appear to come mainly from stronger initial solving rather than better iterative refinement: on IMO-AnswerBench the improvement over the base is +12.0 at single pass but +10.2 at loop 3, i.e., the trained model gains less from looping than the base model.

  2. Only marginal accuracy and diversity distributions are matched (Fig. 12), and results are sensitive to the matching: under accuracy-only control Loop-4 is ~5 points below Loop-3 despite similar diversity (Table 4).

  3. Missing feedback ablations and matched PrefixRL[1]/RSA[2] baselines limit attribution and novelty assessment.

  4. End-to-end training costs are incomplete, while differing scaffolds and evaluation protocols limit efficiency and leaderboard claims.

[1] A. Setlur, Z. Wang, A. Cohen, P. Rashidinejad, and S. M. Xie, "Reuse your FLOPs: Scaling RL on hard problems by conditioning on very off-policy prefixes," in Proc. 43rd Int. Conf. Mach. Learn. (ICML), 2026. [Online]. Available: https://openreview.net/forum?id=a5itZI3DeQ

[2] S. Venkatraman, V. Jain, S. Mittal, V. Shah, J. Obando-Ceron, Y. Bengio, B. R. Bartoldson, B. Kailkhura, G. Lajoie, G. Berseth, N. Malkin, and M. Jain, "Recursive self-aggregation unlocks deep thinking in large language models," arXiv preprint arXiv:2509.26626, 2025.

Questions for authors
  1. Can you provide full accuracy–compute curves and correction/regression rates for matched RL baselines?

  2. How much benefit comes from teacher feedback versus context selection, and how does LoopRL compare with matched prior methods?

  3. What are the total data-generation and training costs, and do the advantages persist under a common scaffold and grading protocol and were training problems decontaminated against these benchmarks?

3 comments
AuthorsOpenReview ↗

Response to Reviewer SWyb

Thank you for the comments. We trained Qwen3-4B on the same LoopRL’s selected contexts after removing their feedback. At inference time, this variant directly revises or aggregates its previous solutions, whereas standard LoopRL also has the evaluated model generate feedback. The two models reach 79.33% and 79.32% mean accuracy. These results indicate that context selection is the main source of LoopRL’s gains. Appendix B.8 reports all scores alongside the solution-only training curves. We also added a comparison of QED-Nano and both LoopRL models under our feedback scaffold, with loop-specific accuracy and effective PFLOPs in Appendix B.9.

PrefixRL. We checked the PrefixRL paper, the first author's publication page, GitHub, and Hugging Face. Amrith Setlur's ars22 account hosts five public checkpoints with names beginning with pope or popemix. We could not verify which, if any, corresponds to the final experiments reported in the paper, so we do not report a matched PrefixRL run.

RSA and QED-Nano. QED-Nano uses the RSA inference scaffold [1,4]. On IMO-AnswerBench, its authors report 76.5% with RSA and 67.5% for QED-Nano alone (Table 1 in [4]). We therefore compare directly with QED-Nano using RSA as our aggregation baseline. In our evaluation, we run the generation and aggregation stages. Both QED-Nano and LoopRL-Qwen3-4B reach 76.4% mean candidate accuracy, at 64.64 and 33.21 PFLOP, respectively.

W1 / Q1: LoopRL improves from 63.8% at loop 0 to 74.3% at loop 3, while the base improves from 51.8% to 64.1%. Accuracy gains are nonlinear: additional loops face increasingly persistent errors, and recursive aggregation can saturate [1,2]. More directly, Figure 5 shows that the base remains below LoopRL's loop-2/loop-3 performance even at loop 15. LoopRL combines stronger initial solving with effective iterative inference.

For sequential refinement on HMMT and AIME, we track each candidate across consecutive inference loops. The correction rate is the percentage of previously incorrect candidates that become correct. The regression rate is the percentage of previously correct candidates that become incorrect. On IMO-AnswerBench, these candidate-level rates are unavailable for models. Each new candidate aggregates three candidates from the preceding loop, so it has no unique predecessor against which to score a correction or regression.

modelbenchmarkloopcorrection rate percentregression rate percent
LoopRL-Qwen3-4BHMMT Nov 20250→133.331.61
LoopRL-Qwen3-4BHMMT Nov 20251→210.261.49
LoopRL-Qwen3-4BHMMT Nov 20252→313.161.98
LoopRL-Qwen3-4BAIME 20260→127.501.50
LoopRL-Qwen3-4BAIME 20261→29.381.92
LoopRL-Qwen3-4BAIME 20262→327.272.42
LoopRL-Qwen3-4BHMMT Feb 20260→118.695.10
LoopRL-Qwen3-4BHMMT Feb 20261→213.682.96
LoopRL-Qwen3-4BHMMT Feb 20262→317.242.82
LoopRL-Qwen3.5-4BHMMT Nov 20250→133.330.51
LoopRL-Qwen3.5-4BHMMT Nov 20251→212.902.39
LoopRL-Qwen3.5-4BHMMT Nov 20252→36.250.96
LoopRL-Qwen3.5-4BAIME 20260→123.811.37
LoopRL-Qwen3.5-4BAIME 20261→215.790.45
LoopRL-Qwen3.5-4BAIME 20262→35.880.45
LoopRL-Qwen3.5-4BHMMT Feb 20260→114.100.54
LoopRL-Qwen3.5-4BHMMT Feb 20261→27.350.51
LoopRL-Qwen3.5-4BHMMT Feb 20262→310.941.50

W2: Table 4 motivates controlling diversity alongside accuracy. With both marginal distributions matched in Figure 3b, accuracy rises from 72.8% at Loop-0 to 81.1% at Loop-4. Joint matching across depths leaves very few usable contexts, so we match the marginals separately and retain 1,628 contexts per arm.

W3 / Q2: We add an experiment for comparing solution-only and solution-plus-feedback training (Appendix B.8). Both variants train on the same selected questions and stored solutions. Standard LoopRL (solution-plus-feedback) also conditions on stored feedback, whose tokens are excluded from the policy loss. At inference it generates its own feedback, while the solution-only model revises or aggregates its previous solution directly. Standard LoopRL scores higher on AIME 2026 and IMO-Answerbench, and the solution-only variant scores higher on both HMMT benchmarks. With selected contexts, solution-only reaches 79.33% versus 79.32% with feedback (Table 5). Figure 4 additionally demonstrates the selection benefit on the same questions. These results indicate that context selection is the main source of LoopRL’s gains; explicit feedback provides no gain in mean accuracy.

Our contribution is the systematic study of RL on loop data: solution diversity, loop count, context topology, and context selection. These ablations yield the latest-eligible-state selection rule, reaching the IMO gold medal level for 4B model by training on the selected loop contexts.

W4 / Q3: The final Qwen3-4B RL run uses 1,632 H200 GPU-hours. Inference overhead is reported in Figure 5. Data generation uses 64,920 PFLOP in total, and the collected data are reused for both model families. We ensure that the training data are decontaminated against all evaluation benchmarks.

We additionally evaluated QED-Nano with our feedback scaffold and reported all five loops in Appendix B.9, Table 7. It achieves 76.19% at 57.85 effective PFLOPs, versus 76.44% at 33.21 for LoopRL-Qwen3-4B and 82.50% at 42.81 for LoopRL-Qwen3.5-4B. These models give accuracy gains of 0.25 and 6.31 points with 42.6% and 26.0% less effective compute, respectively.

In conclusion, we systematically studied which data from multi-loop reasoning trajectories are most useful for RL training, and proposed the data selection method from the experiments. Training on the selected 5.2K contexts brought a 4B model to the IMO gold medal level. The 4B model reaches 82.5% on IMO-AnswerBench, above the reported 80.0% score of Gemini Deep Think (IMO Gold) on that benchmark. We release all training code and data to enable reproduction and further study of RL on feedback loops.

[1] Venkatraman et al. Recursive Self-Aggregation Unlocks Deep Thinking in Large Language Models. Section 5.4. https://arxiv.org/abs/2509.26626v2

[2] Snell et al. Scaling LLM Test-Time Compute Optimally can be More Effective than Scaling Model Parameters. Section 6. https://arxiv.org/abs/2408.03314

[3] Setlur et al. Reuse your FLOPs: Scaling RL on Hard Problems by Conditioning on Very Off-Policy Prefixes. Section 5. https://arxiv.org/abs/2601.18795v2

[4] Qu et al. QED-Nano: Teaching a Tiny Model to Prove Hard Theorems. Appendix B. https://arxiv.org/abs/2604.04898

Thank you for the ablations and the comparison with QED-Nano. I still have three concerns. First, I would like to see how LoopRL compares with RL baselines on correction and regression rates. Second, it remains unclear whether LoopRL can improve a stronger initial solver. Third, matching accuracy and diversity alone does not isolate the effect of loop depth. I therefore keep my rating at 2.

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