1. The benchmark subset changes substantially, and comparability is unresolved
Section 3.1 states that preprocessing reduces the usual 100,000 training pairs to 14,770, and the 100 test pairs to 52, because some PDB files cannot be converted into hypergraphs. This removes 85.23% of training examples and 48% of test examples. Such extensive filtering can materially change both the training problem and the difficulty of the test set.
Were all baseline results in Table 1 recomputed on these exact 52 pockets using the same evaluation pipeline, or were some taken from published results on a different subset? The manuscript does not make this clear. Until it does, the reported ranking cannot be interpreted confidently. Please release the retained identifiers, exclusion reasons, and evaluation outputs, and compare the retained and excluded pockets in size, target family, and ligand properties. If practical, repair the parser and report performance on the full standard test set.
The ChEMBL pretraining overlap also needs to be audited. Report exact-compound and scaffold overlap with test ligands, as well as target/pocket similarity across the supervised split. CrossDocked contains multiple poses and related structures; counting pairs does not establish the number of independent proteins or ligands. These are requests for a data audit, not an allegation of leakage.
2. The numerical results do not yet establish a robust improvement
The leading docking comparison is −7.693 versus −7.642, an absolute difference of 0.051 kcal/mol (Table 1). Presenting this as a 0.67% improvement gives an impression of precision without showing uncertainty or practical relevance. No per-pocket confidence intervals or independent-run variability are reported. The full model also has lower QED than TSMGen, 0.606 versus 0.659, and ties its normalized SA at the precision shown in Table 1.
Table 2 further weakens the claim that the proposed components are necessary for better target binding. Removing the atom graph improves docking from −7.693 to −7.708; removing both BCF and AGMF improves it to −7.730. Removing the hypergraph changes docking by only 0.002. The QED improvements of the full model are more consistent, but modest. This supports a possible trade-off, not a clear overall superiority claim.
Please report paired per-pocket differences, uncertainty across training and sampling seeds, and a prespecified multi-metric success criterion. For generalization across targets, the pocket—not each sampled molecule—should be the primary unit of statistical comparison.
The additional results in Table 3 compare the best docking score with different baselines on different targets. These values depend strongly on how many candidates were generated and how they were selected. They cannot substitute for a common all-method/all-target evaluation with a matched sampling budget.
3. Several method definitions are inconsistent or undermine the proposed interpretation
The hypergraph is defined in two incompatible ways. Section 2.2 constructs edges using the minimum heavy-atom distance between residues below 5 Å. Appendix A.2 instead uses Cα–Cα distances below 5 Å. These produce different neighborhoods: side-chain contacts can be close while their Cα atoms are much farther apart. Please state which definition was implemented and update the other description.
The interaction block does not explicitly transmit neighboring atom features as written. In Equations (21)–(23), the key and value for edge (i,j) are computed from [hi,eij], while Equation (20) defines the edge feature from distance. There is no hj in this message. With these definitions, an update can depend on the central atom and surrounding distances without directly knowing the chemical identity of the atom at the other end of each edge. This matters for distinguishing, for example, different chemical partners at comparable distances. Is Equation (21) meant to contain hj, or is there an omitted edge update or chemical edge feature? If the implementation follows the printed equations, the claim of learning chemically specific interaction patterns needs stronger support.
The “reverse” fusion matrix contains the same information as the forward matrix. Equations (9)–(10) give Mf=ah⊤ and Mr=ha⊤=Mf⊤. Flattening the transpose simply permutes the entries. Separate learned projections can provide extra capacity, but they do not by themselves establish a new directional interaction mechanism. A parameter-matched single-outer-product control is needed to support that interpretation.
The cross-attention description needs tensor-level clarification. The pocket encoders are globally pooled to one vector per example, and the generator uses pocket features as keys and values. If this is one key/value token per pocket, the attention softmax is identically one and that branch cannot select pocket information based on the molecular query. If the vector is expanded into multiple tokens, or unpooled features are used, please specify how. The reverse branch also needs a clear description of causal masking during training.
Some of these issues may be typographical or omitted implementation details. They should be resolved rather than treated as demonstrated implementation bugs. Together, however, they make it difficult to assess the method's central technical claims.
4. The contribution of interaction supervision and fusion is not isolated
The paper combines established ingredients: pretrained sequence embeddings, graph/hypergraph encoders, jumping-knowledge aggregation, contrastive alignment, bilinear feature interactions, gates, and a conditional language model. Such an integration can be useful, but the novelty needs to be located precisely and supported by controlled evidence.
TSMGen is an especially relevant comparator: it is cited as a method based on higher-order structural dependencies and bidirectional fusion, yet the paper does not explain clearly what CoPocket changes relative to it beyond the aggregate performance table. A component-level comparison would be more informative than a list of separately named modules.
Please include a generator with the same ChEMBL pretraining and training budget but a simple pooled pocket representation, a parameter-matched concatenation/bilinear fusion baseline, and shuffled-pocket or mismatched-pocket controls. The latter are important because favorable QED, SA, and pooled diversity can come from the molecular prior even if the model uses little target information.
The contrastive negatives also need attention. Equations (3)–(5) treat all off-diagonal pocket–interaction pairs as negatives. Repeated pockets with different valid ligands can therefore create contradictory supervision. Please describe grouping, deduplication, and multi-positive handling. Distinguishing correct from perturbed poses of the same pocket–ligand pair would more directly test whether the representation learns interactions rather than pocket identity.
5. The geometry, efficiency, and molecular-quality comparisons lack an end-to-end protocol
Appendix A.4 describes a SMILES generator, but the paper then evaluates bond lengths, all-atom distances, docking poses, and generation speed against methods that generate 3D structures directly. The conversion from generated SMILES to coordinates is not adequately specified. If a conformer generator or force-field optimization determines bond lengths, the agreement in Figure 2 cannot be attributed solely to CoPocket learning geometry.
Please document the full pipeline: SMILES sanitization, stereochemistry, conformer generation, minimization, protonation, receptor preparation, docking settings, and rejected samples. This is particularly important because the preprocessing mentions “isomer removal” without defining whether it means removing stereochemical information or eliminating duplicate stereoisomers.
Similarly, 4.3 seconds for 100 molecules in Figure 7 is encouraging, but only comparable if all methods are timed to the same output: for example, valid molecules with usable 3D conformers, or docked candidates. Separate decoding, conformer generation, and docking time, and report common hardware, batching, and success counts.
The main table omits validity, uniqueness, and explicit training-set novelty, which are important for an autoregressive SMILES model. Although Section 3.3 gives the SA range as 0–1, please provide the normalization formula, the diversity fingerprint/distance, and the precise Lipinski definition. The latter is described as a count of conforming molecules, while the table reports values around 4–5, suggesting a different quantity such as the average number of satisfied criteria. A t-SNE plot cannot establish novelty or broad chemical-space coverage by itself.
6. The case-study interpretation exceeds the evidence and contains inconsistencies
Docked poses and distances of 2.2–3.4 Å do not establish stable hydrogen bonds or robust binding, as claimed in Section 3.6. Hydrogen-bond assignment also depends on donor/acceptor chemistry and geometry. Appendix A.6 assigns multiple hydrogen bonds to aromatic fluorine and a halogen bond to fluorine; these assignments require particular care and should not be inferred from contact proximity alone.
There is a concrete consistency problem in the Mol_1 discussion: Appendix A.6 refers to a “phenyl ring connected to the cyano group,” but the Mol_1 SMILES in Figure 3 contains a trifluoromethyl group and no nitrile. The Mol_1 structure in the Figure 9 interaction diagram also appears different from the structure in Figure 3. Please reconcile molecule identities, poses, interaction diagrams, and prose using a single set of deposited structures and identifiers.
Finally, 7KZH and 7TGQ are structures of the PARP13/ZAP central domain, not independent protein targets. The paper correctly introduces them as PARP13 structures, but the concluding language about validation “across different targets” overstates the breadth of this case study. Docking candidates to these structures is a useful hypothesis-generation exercise; it does not establish target specificity or biological modulation.