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Under review as a conference paper at ICLR 2027

Execute–Verify–Commit: Action-level Verification for Long-Horizon Agents

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Abstract

In long-horizon tasks, a tool call can execute successfully while making a change that violates the user's instructions or the environment's operating rules. Such changes may compound across subsequent actions and leave the environment in a state that is difficult to recover from, causing the agent to spend its remaining steps on unsuccessful retries. We introduce Execute–Verify–Commit (EVC), a training-free method for action-level review before state changes are committed to the live environment. EVC executes a proposed state-changing action in an isolated fork and reviews the resulting tool output and state changes against user instructions and applicable policies, using the interaction history as context. Approved changes are committed without re-executing the action; rejected changes are discarded, and a specific explanation guides the agent's next step from the unchanged live state. With a fixed LLM reviewer and one review per candidate action, EVC improves average task success over no-review baselines across three top-tier acting LLMs-Qwen3.8-max, GLM-5.2, and Kimi-K3-on three benchmarks. Further experiments show benefits from execution evidence and specific rejection feedback, with little consistent gain from repeated voting. The discriminative reviewer Jev offers lower per-review cost but lower task success than the Qwen reviewer.

Primary area:
foundation or frontier models, including LLMs
Keywords:
large language model agents, long-horizon tasks, tool use, action-level verification, execution feedback

Reviews

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1234this paper, Top 15%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_t2SyOpenReview ↗
Rating
3(+1)
Confidence
3
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper introduces Execute-Verify-Commit (EVC), which is a training-free wrapper for state-changing agent tool calls. It executes each candidate call in an isolated environment fork, exposes tool output and state differences to an LLM reviewer, and promotes the reviewed fork to live state without re-executing the call if approved. Rejected candidates are discarded and generate feedback. Evaluation uses three acting models on τ-bench, τ², and STATE-Bench, with four runs per task.

Critical strengths
  1. The paper targets a concrete and under-studied failure mode: a tool call can silently change the environment state, even when it returns an error, so the agent keeps acting on a corrupted state and wastes its remaining budget on futile retries. This angle is clearly distinct from prior work. Pre-execution checks see only the call, not its actual effects, and post-trial reflection steps in only after the episode, when the state is already corrupted. This failure mode matters in practice for long-horizon, stateful agents.
  2. EVC is a simple, training-free wrapper with a clean execute → verify → commit structure. It leaves the agent's planning loop untouched and works with different models. The reviewer judges the effects that the action actually produces in an isolated fork, not effects predicted by a model. On approval, the reviewed state itself is committed, so what was reviewed is exactly what takes effect. On rejection, the live state is preserved, and the agent can revise its action using specific feedback. Ablations confirm that both the execution evidence and the specific feedback contribute.
Critical weaknesses
  1. The paper never measures how accurate the reviewer's judgments are, so the mechanism itself is not directly validated. The paper reports only final task success, with no reviewer-level statistics: the rejection rate, the false-rejection rate, the fraction of harmful changes that were blocked, and the number of episodes that ended after repeated rejections are all missing. The appendix itself notes that its failure cases "motivate measuring false rejections," yet the paper does not do so. τ-bench and τ² provide reference action sequences, and all three benchmarks have deterministic state checks, so each reviewed candidate could be labeled as consistent or inconsistent with the reference trajectory and rejection precision and recall reported. Without these numbers, readers cannot tell whether the modest gains come from blocking harmful writes, as the paper claims, or from side effects such as the extra turns after a rejection changing the conversation with the user simulator. The authors should at least report per-benchmark rejection rates, along with rejection precision and recall measured against the reference trajectories.
  2. Using Qwen3.8-max as user simulator, outcome judge, and reviewer may confound the main gains. The same model simulates the user, scores the language-based requirements in τ² and STATE, and serves as the "common" reviewer. The paper itself attributes its clearest gains to communication behaviors such as asking for clarification, and these are exactly what the Qwen judge scores. A Qwen reviewer may therefore steer the acting agent toward dialogue behavior that Qwen prefers and inflate Qwen-judged scores without the task actually being done better; the Jev-versus-Qwen comparison is exposed to the same issue. The authors should re-score with a different judge model or report state-only success rates, and add a cross-family reviewer for the Qwen acting agent.
Questions for authors
  1. What rejection, false-rejection, repeated-rejection termination and caught-harm statistics are available? Which tool effects are genuinely isolated by the fork implementation, and what end-to-end fork/commit overhead was measured?
  2. What are the exact task denominators and exclusion rules for each actor and condition? Were all review conditions evaluated on the same task subset, and which failures or API/context errors were excluded?
6 comments
AuthorsOpenReview ↗

Responses Part1

W1&Q1(1): We added a fine-grained audit of individual review decisions, which demonstrates that our method effectively catches nearly all harmful actions with high recall, while also highlighting the need to further improve verification precision.

What rejection, false-rejection, repeated-rejection termination and caught-harm statistics are available?

τ-bench and τ² provide reference action sequences, and all three benchmarks have deterministic state checks, so each reviewed candidate could be labeled as consistent or inconsistent with the reference trajectory and rejection precision and recall reported.

The authors should at least report per-benchmark rejection rates, along with rejection precision and recall measured against the reference trajectories.

Thank you for highlighting this critical gap. We fully agree that final task success alone is insufficient to establish the reliability of individual review decisions. To address this, we conducted a fine-grained, model-assisted audit across all 242 outcome-changing task–seed runs (148 rescues and 94 harms). This audit covers Qwen3.8-max, GLM-5.2, and Kimi-K3 acting agents paired with a Qwen3.8-max B1 reviewer across three benchmarks and four seeds, utilizing the more capable GPT-6.1-Sol as the auditor.

Methodology Justification: We carefully considered your suggestion to use reference-trajectory agreement or deterministic terminal-state checks to evaluate action validity. However, we opted for a context-aware model audit for two reasons: (1) reference sequences rarely exhaust all legitimate intermediate behaviors, and merely matching an action type does not guarantee that its parameters and user authorizations are appropriate for the current dynamic interaction; and (2) terminal-state checks evaluate final task completion rather than the step-level validity of intermediate actions. Therefore, we instructed GPT-6.1-Sol to evaluate candidate actions directly against the policies, tool requirements, user authorizations, and staged effects available at the exact moment of the review decision.

Metrics & Results: Treating actions audited as “should be rejected” as the positive class, we report the Rejection Rate (observed fraction of candidates rejected), False-Rejection Rate (FP/(FP+TN)\text{FP}/(\text{FP}+\text{TN})), Rejection Precision (TP/(TP+FP)\text{TP}/(\text{TP}+\text{FP})), and Recall / Caught-Harm Rate (TP/(TP+FN)\text{TP}/(\text{TP}+\text{FN})):

Table 1. Review reliability metrics and repeated-rejection statistics across 242 audited runs.

BenchmarkRejection rateFalse-rejection rateRejection precisionRecall/Caught-harm RateEpisodes with $\ge$2 rejectionsLimit endings (failed)
τ\tau-bench53.06%34.85%55.77%90.62%173 (2)
τ2\tau^256.07%41.24%45.52%98.39%214 (4)
STATE44.15%30.41%44.79%96.05%322 (2)
Overall49.82%34.55%47.88%95.05%709 (8)

Analysis of Repeated Rejections: Here, repeated rejection refers to episodes with at least two actual rejections. Out of 70 such episodes, 37 ultimately succeeded and 33 failed. Only nine episodes terminated due to reaching a step, error-count, or tool-round limit; among these, eight failed, while one still satisfied the benchmark outcome checks. This shows that agents can often learn and recover from multiple rejections without running out of steps.

Discussion & Takeaway:

  1. High Recall in Blocking Harm: The reviewer demonstrates strong safety efficacy, achieving a 95.05% overall caught-harm rate.

  2. Precision vs. Baseline: While the 47.88% precision and 34.55% false-rejection rate indicate a conservative bias, this should be contextualized against the base rate: only 25.03% of assessable candidates in this audit were genuinely rejectable. A random, risk-agnostic rejection baseline would yield an expected precision of 25.03%. Our reviewer achieves 47.88%, representing an approximate 1.91-fold risk enrichment.

In summary, these results confirm that our current review mechanism is highly effective at intercepting harmful actions, though it remains conservative when recognizing valid alternative intermediate steps. In future work, we plan to reduce unnecessary rejections by improving rejection calibration, training reviewers with explicit positive examples of valid intermediate actions, and enhancing the accuracy of corrective feedback.

AuthorsOpenReview ↗

Responses Part2

W2:We clarify that EVC’s gains stem from concrete operational corrections (e.g., valid database states) rather than stylistic communication preferences. Furthermore, we added two cross-model control experiments—swapping the outcome judge and swapping the action reviewer across different model families—confirming that EVC's improvements consistently hold regardless of model pairings.

The paper itself attributes its clearest gains to communication behaviors such as asking for clarification, and these are exactly what the Qwen judge scores. A Qwen reviewer may therefore steer the acting agent toward dialogue behavior that Qwen prefers and inflate Qwen-judged scores without the task actually being done better; the Jev-versus-Qwen comparison is exposed to the same issue.

The authors should re-score with a different judge model or report state-only success rates, and add a cross-family reviewer for the Qwen acting agent.

We thank the reviewer for raising this important concern. While our discussion of user clarification in STATE shopping (Section 4.2) might have given the impression that the gains primarily reflect stylistic or communication preferences, our case studies demonstrate that improvements largely stem from concrete operational corrections. These include fixing action ordering, preventing state changes that block subsequent operations, and preserving actionable tool-error information. For instance, in τ-bench retail task 98, EVC prompts the agent to update the shipping address before replacing an item, thereby preventing an order lock. This success directly reflects a valid final database state rather than a more favorably judged conversation.

Nevertheless, we agree that keeping the outcome judge fixed does not, by itself, fully rule out shared-model bias. We therefore conducted two cross-model control experiments using Qwen3.8-max as the acting agent.

Control 1: Swapping the Outcome Judge. First, we replaced the language-based outcome judge, re-scoring the exact same trajectories with GLM-5.2 and Kimi-K3 while keeping the Qwen action reviewer, trajectories, and deterministic checks fixed.

Table 1. Outcome-judge controls on the original full task panels. Each cell reports baseline → EVC Avg@4 (%), followed by the gain in percentage points.

Outcome judgeτ²STATE
Qwen3.8-max, original82.73 → 83.27 (+0.54)56.83 → 58.67 (+1.83)
GLM-5.282.82 → 83.36 (+0.54)59.00 → 61.00 (+2.00)
Kimi-K382.73 → 83.27 (+0.54)58.33 → 60.33 (+2.00)

We exclude τ-bench from this control because its deterministic outcome evaluation does not involve an LLM judge. For τ² and STATE, we re-score the same baseline and EVC trajectories using GLM-5.2 and Kimi-K3. Baseline scores differ because judges can disagree on whether the same trajectory satisfies the language-based requirements; neither the trajectories nor the deterministic state checks change. Each gain is therefore computed against the baseline scored by the same judge. Judge choice introduces little variation in the estimated gains: the improvement remains 0.54 percentage points on τ² and ranges from 1.83 to 2.00 points on STATE. These results show that EVC's positive gains persist beyond Qwen-based outcome evaluation.

Control 2: Swapping the Action Reviewer. Second, we replaced the action reviewer with GLM-5.2, Kimi-K3(all using one verification step per candidate), while keeping Qwen3.8-max as the acting agent and outcome judge.

Table 2. Action-reviewer comparison with Qwen3.8-max acting and outcome judging. Each cell reports Avg@4 (%) and the increase compared to the no-review baseline in percentage points.

Action reviewerτ-benchτ²STATE
No review60.1582.8256.83
Qwen3.8-max61.52 (+1.36)83.27 (+0.45)58.67 (+1.83)
GLM-5.262.27 (+2.12)83.09 (+0.27)58.00 (+1.17)
Kimi-K365.00 (+4.85)86.45 (+3.64)58.33 (+1.50)
Jev57.73 (−2.42)73.55 (−9.27)55.17 (−1.67)

Across all three LLM reviewers (Qwen3.8-max, GLM-5.2, and Kimi-K3), every configuration consistently outperforms the no-review baseline across all three benchmarks. In contrast, Jev falls below the baseline on all three benchmarks (−2.42, −9.27, and −1.67). This demonstrates that the positive effect of EVC does not rely on a specific LLM family serving as the reviewer (nor on reviewer–judge self-preference), whereas a reviewer that merely returns fixed categorical feedback rather than task-specific explanations fails to yield the same benefit.

AuthorsOpenReview ↗

Responses Part3

Q1(2):We detail our state isolation mechanisms (Table 1) and commit protocols, showing how state copying and request staging prevent premature side effects.

Which tool effects are genuinely isolated by the fork implementation

State Isolation & Commit Mechanisms: In our design, environment adapters isolate the side effects of candidate actions—covering both benchmark database records and internal tool states—by executing actions on separate, isolated copies of the state. This guarantees that the live environment remains completely unchanged until the action is approved. Table 1 summarizes our implemented isolation mechanisms alongside a practical extension for external services via request staging (with detailed commit conditions provided in Appendix F.1).

Table 1. Isolation mechanisms for benchmark state and external-service extensions.

State or effectConcrete examplesIsolation mechanism
Benchmark database recordsOrders, bookings, addresses, carts, balances, and simulated refund or compensation recordsDirect: candidate tools update copied records without changing the live records before approval.
Internal tool stateWhether a return or refund has been previewed, or a required policy has been checkedDirect: τ²/STATE copy these states as part of the environment object, so candidate changes remain within that copy until approval.
Requests to external servicesA real payment request or an email to be sentIndirect, through request staging: an external-service adapter would hold the request in a staging area, send it only after approval, and remove it on rejection.

Depending on the nature of the action, commit and rejection are handled in two ways:

  • Local Benchmark & Tool States (Direct Copy): The adapter commits the reviewed state copy only if the live environment has remained unchanged since staging, thus avoiding redundant tool re-execution. If rejected, the candidate copy is simply discarded, leaving the live state untouched.

  • Irreversible External Services (Request Staging): For real-world external actions (e.g., processing a live payment or sending an email), the staging extension intercepts and holds the outbound request in a buffer until approval. If approved, the request is dispatched; if rejected, the pending request is simply dropped from the buffer—eliminating the need to undo an already executed payment or recall a delivered message.

Q1(3):Expanding on Appendix B.4, we added a component-wise latency breakdown across 11,245 transactions, showing that EVC incurs modest overall latency (mainly from LLM inference) while local state forking and committing add negligible overhead.

what end-to-end fork/commit overhead was measured?

End-to-End Verification Latency Breakdown: While Appendix B.4 and Figure 7 already report reviewer token usage, request latency, and API-cost estimates, we now supplement these results with a granular component-wise latency breakdown across 11,245 recorded verification transactions from 5,549 runs spanning all three benchmarks. Each transaction encompasses the complete lifecycle of a review: the forked execution of a candidate action (or tool batch), the reviewer's evaluation, and the final state commit or discard. Across all three acting models, Qwen3.8-max serves as the B1 reviewer (reviewing budget = 1).

Table 2. End-to-end verification latency breakdown by component and acting model (s; transaction-level means, pooled P95).

ComponentQwen actingGLM actingKimi-K3 acting
Transactions3,9823,5833,680
Forked execution and evidence construction0.22430.20210.7771
Reviewer evaluation2.41082.72153.5414
Local checks and commit/discard0.04140.04020.2032
Total verification time2.67652.96384.5217
P95 total time3.93884.27939.9562

Here, Reviewer evaluation covers prompt preparation, LLM decision generation, and response parsing, while Local checks and commit/discard includes evidence validation, local runtime operations, and committing or discarding the candidate state.

As shown in Table 2, the total verification latency is modest—averaging only a few seconds per transaction—with the Reviewer evaluation accounting for the vast majority (78%–92%) of the elapsed time, whereas local state forking and commit/discard operations take well under a second. Overall, these results confirm that EVC enhances reliability on long-horizon tasks with very manageable latency overhead.

Reviewer_6tjAOpenReview ↗
Rating
3(+1)
Confidence
3
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

This paper proposes Execute-Verify-Commit (EVC), a training-free framework for action-level verification and recovery. EVC isolates candidate actions, uses an LLM to review actual effects against constraints, and either commits or discards them with corrective feedback. Key contributions include: i) a state-preserving verification mechanism; ii) evidence that a single Qwen reviewer improves task success across multiple models in long-horizon tasks; and iii) analysis showing that observing actual effects with specific rationales outperforms mere blocking or repeated reviews. Experiments on policy-constrained benchmarks demonstrate that EVC consistently improves task success and multi-run consistency compared to no-review and self-review baselines.

Critical strengths
  1. The paper addresses an important reliability issue in long-horizon agents: tool actions may fail or violate constraints despite appearing appropriate at the decision level.

  2. EVC combines isolated execution, verification of actual effects, and commit-or-discard semantics, offering a practical approach to preventing rejected actions from altering committed state.

  3. The paper evaluates multiple acting models across several benchmarks and includes ablations on execution evidence and corrective feedback, providing useful insights into the framework's effectiveness.

Critical weaknesses
  1. EVC assumes that candidate actions can be safely executed in isolation and their resulting states committed. How does it handle irreversible external side effects and ensure that the reviewed state remains consistent with the real environment?

  2. The current comparisons with no-review and self-review baselines do not isolate the incremental benefit of EVC's execute–verify–commit mechanism. Could the authors compare EVC against a dialogue-grounded pre-execution verifier using the same reviewer, acting agent, feedback allowance, and task budget?

  3. The paper does not directly evaluate the reliability of the LLM reviewer. Could the authors quantify false acceptance and false rejection rates, particularly how often valid actions are incorrectly blocked and whether such rejections harm task completion?

  4. The operational cost and failure modes of EVC remain insufficiently characterized. Could the authors report end-to-end latency and cost, including adapter overhead, and analyze the causes of harmful interventions in Table 7? For Table 4, how were recoverable first-rejection cases selected, how many were excluded, and was selection independent of subsequent outcomes?

Questions for authors

See weaknesses.

Reviewer_vgHXOpenReview ↗
Rating
3
Confidence
2
Informativeness
3
Presentation
2
Soundness
2
Read review
Paper summary

This paper addresses error propagation in multi-step tool interactions, where an improper state modification can prevent subsequent operations from being completed. The authors propose EVC (Execute–Verify–Commit), which executes actions in an isolated environment and then determines whether to commit the changes based on the interaction history, predefined rules, and actual execution outcomes. If approved, the reviewed state is committed directly without re-executing the action; otherwise, the candidate changes are discarded and corrective feedback is provided. The approach requires no model retraining. The method is evaluated across three acting models and three benchmarks, with analyses of the effects of execution outcomes, rejection feedback, and the number of reviews per action.

Critical strengths
  1. The paper addresses a well-defined problem with a practical solution. Tool outputs, whether success signals or error messages, do not always fully reflect the actual changes made to the environment. EVC verifies these changes before deciding whether to commit them. By preserving the original live state when an action is rejected, it gives the agent an opportunity to adjust its subsequent actions. The workflow in Section 3.2 and the examples in Appendix E clearly illustrate the utility of this design. For environments that support isolated execution and state commitment, EVC provides an additional verification layer for existing agents without requiring training.

  2. The evaluation covers a broad range of models and benchmarks, and the analysis of feedback mechanisms is valuable. The authors evaluate the method across multiple models and benchmarks, reporting both improvements and degradations in task performance resulting from verification. Section 4.3.2 compares the effects of generic rejections and specific, explanatory feedback on subsequent performance, starting from the same first-rejection point. Although these results are based on a selected subset of samples, the comparison helps illustrate that explaining what went wrong may help the agent complete the task, beyond preserving the opportunity to retry.

Critical weaknesses
  1. The additional value of verification after execution, compared with verification before execution, remains somewhat unclear. In Section 4.3.1, the authors remove actual execution outcomes from the verifier's input while retaining the original verification prompts. As shown in Appendix D, these prompts explicitly instruct the verifier to inspect execution results and reject actions when evidence is insufficient. This setup therefore does not provide a direct comparison with a verifier designed specifically to use information available before execution. Although the ablation demonstrates the utility of execution outcomes within the current framework, I would still like to see a comparison with a well-designed verifier operating before execution to assess the additional value of trial execution.

  2. The analysis of long-range error propagation could be more direct. The verifier has access to the interaction history, and Appendix E provides examples of adjusting the sequence of operations in advance to prevent subsequent tasks from being blocked. However, the overall results in Section 4.2 and Appendix B do not establish what proportion of the gains comes from correcting parameter or rule-based errors in the current action, versus preventing downstream issues. A breakdown of successful and failed cases, particularly those requiring multi-step historical context to assess risk, would better illustrate the specific scenarios in which the method is effective.

  3. The scope of the evaluation and certain comparative results require further clarification. In Appendix B.2, the number of tasks evaluated for Kimi is smaller than the scale indicated in Section 4.1 and Appendix A.1, and the criteria used to select these tasks are insufficiently explained. This makes it difficult to determine which tasks are covered and whether the excluded tasks share common characteristics. Furthermore, as noted in Section 4.2 and Appendix B.3, the comparison involving "Jev" changes both the reviewer model and the feedback format. These results therefore support a comparison of the overall configurations but cannot isolate which model is better at determining whether an action is correct.

Questions for authors
  1. Could you include a control condition in which the verifier uses only information available before execution? Please keep the acting model, reviewer model, number of verification steps, and feedback format constant, while adjusting the verification prompts accordingly.

  2. Can existing logs distinguish corrections to the current action from interventions that prevent subsequent tasks from being blocked? Please also identify any cases in which the information available at the time was sufficient to detect a risk, but the risk remained unidentified.

  3. What selection and exclusion criteria were used for the subset of tasks actually evaluated? Please also clarify how missing runs were handled and whether both sides of each comparison used the same set of tasks.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Summary of discussion and many thanks.

Throughout the discussion, we have addressed concerns about the implementation scope, experimental fairness, evaluation consistency, and reviewer reliability. Specifically, we clarified the isolation boundary and commit conditions; added a tailored pre-execution verifier and cross-family reviewer and outcome-judge controls; corrected task denominators and aggregation issues; and expanded the decision-level audits, independent auditor validation, failure analysis, and verification-cost reporting. We also clarified the selection protocol for the first-rejection experiments and the limitations of our findings. We have submitted a revised manuscript incorporating these additional experiments and analyses into the main text and appendices, with changes highlighted in green. We sincerely thank all reviewers and the Area Chair for their time, careful evaluation, and constructive feedback, which have helped us strengthen the empirical evidence and improve the clarity and transparency of the paper.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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