acceptodds
Under review as a conference paper at ICLR 2027

Task-Conditioned Quality Learning for Heterogeneous and Unreliable Multi-Agent Systems

Abstract

We study a heterogeneous multi-agent setting in which any open-world intelligent entity, including AI models, human-operated components, and hybrid systems, can be represented as a callable intelligence node. Such a setting expands the boundary of single-form intelligence, but it is difficult to orchestrate because the internal behavior and ability of nodes are usually not observable, making public descriptions an uncertain guide to actual execution quality. Deceptive profiles and collusive feedback can further distort task allocation. We propose HICS, a Heterogeneous Intelligence Coordination System that serves as an external routing and quality-control framework for such open node pools. HICS adopts a task encoder that learns the task geometry online from previously available feedback and maintains task-conditioned rolling quality expectations, complemented by a direct contextual estimate, to identify which nodes are likely to respond reliably under the current task condition. To facilitate learning, HICS supports separate answering and evaluation roles to obtain denser weak supervision, with reference feedback and audit anchors for calibration. We construct two complementary evaluation settings: a MedAgentBoard-based semi-synthetic medical benchmark for heterogeneous routing under partial outcome feedback, and controlled simulations that examine misleading profiles, hidden specialization, and collusive behavior. Comparisons and ablation studies assess routing quality, quality-model components, and the contribution of weak feedback. The results demonstrate the effectiveness and limits of task-conditioned reliability learning in the evaluated heterogeneous node pools.

Primary area:
applications to computer vision, audio, language, and other modalities
Keywords:
Heterogeneous multi-agent systems;task-conditioned routing;online quality learning;contextual bandits;

Reviews

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1234this paper, Top 49%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.33 over 3 reviews, above 51% of the others.
Reviewer_qbdKOpenReview ↗
Rating
3
Confidence
3
Informativeness
2
Presentation
3
Soundness
3
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Paper summary

The paper introduces HICS (Heterogeneous Intelligence Coordination System), an external routing and quality-control framework for coordinating heterogeneous agents whose actual task-specific performance may differ from their public descriptions and whose feedback may be unreliable. The key idea is to learn each agent’s expected execution quality conditioned on the current task, using historical outcomes and feedback. HICS combines task-similarity-based local quality estimation with a direct contextual predictor to guide agent selection and exploration. It also separates answering from evaluation, maintains distinct estimates of executor and evaluator reliability, and uses reference feedback and labeled audit anchors to calibrate weak evaluations. Feedback is used to improve subsequent routing decisions rather than influence the decision that generated it.

Contributions

  1. Formulating multi-agent coordination around task-specific execution quality, distinguishing public task-fit descriptions from observed performance.
  2. Combining learned task geometry, local rolling quality estimates, direct contextual prediction, exploration, and separate executor/evaluator reliability modeling within HICS.
  3. Incorporating weak evaluations, reference feedback, and audit anchors to improve quality estimates when directly verified outcomes are limited.

Validation

  1. HICS with peer evaluation achieves 75.18% accuracy, outperforming NeuralUCB-Diag (71.80%) across four MedAgentBoard-based datasets.
  2. HICS achieves 73.17% full-stream and 80.92% final-window accuracy, outperforming LinUCB by 9.13 and 7.75 percentage points, respectively. However, full HICS uses additional evaluation requests, limiting the fairness of total-resource comparisons.
  3. Direct contextual prediction provides substantial gains, while online task-geometry learning has minimal impact in the tested simulations.
Critical strengths
  1. The paper addresses a meaningful problem by jointly modeling task-conditioned agent quality and evaluator reliability, recognizing that public agent descriptions may not reflect actual performance and that evaluation feedback can itself be unreliable. This provides a coherent framework for improving agent selection when directly verified outcomes are limited.
  2. HICS outperforms the strongest listed non-privileged baseline in both medical routing and controlled simulations. The ablation studies further identify direct contextual prediction as a major contributor to performance. These results provide empirical support for the framework, although the additional evaluation budget used by full HICS limits the strength of resource-matched comparisons.
Critical weaknesses
  1. Full HICS uses 2640 additional evaluation requests beyond the 7200 answer invocations shared by the compared methods. Consequently, its reported gains over LinUCB do not isolate the benefits of the proposed quality-learning framework from those of additional evaluation resources, weakening the evidence for its overall effectiveness.
  2. The framework relies on weak evaluations to update agent quality estimates, but the main simulations assume evaluators perform above chance and remain independent of answer-role collusion. Without stronger evaluation under coordinated or strategically manipulated evaluators, the paper does not sufficiently establish the reliability of its quality-control mechanism in the unreliable multi-agent settings it targets.
Questions for authors
  1. Can the authors quantify HICS's performance under a matched total interaction budget, including both answer and evaluation requests, to establish whether its gains over existing routing methods persist when resource consumption is controlled?
  2. How sensitive is HICS to evaluator unreliability, particularly when evaluators systematically provide incorrect feedback or collude with answering agents, and what evidence supports the effectiveness of its evaluator-reliability estimation under these conditions?
4 comments
AuthorsOpenReview ↗

1. Comparison under matched interaction budgets (Weakness 1, Question 1)

We apologize for the late response, following our recent CVPR submission. We greatly appreciate your careful review and your recognition of the framework's motivation. We agree that the original comparison combines the learning method with additional evaluation resources. We have therefore added request-matched comparisons with four baselines, using the original task streams, node pools, and GT masks. The complete HICS method is unchanged.

We compare the original baselines, HICS with evaluation removed, baselines augmented with evaluations, baselines given more answerers, and full HICS. The two augmented groups receive the same total number of requests as full HICS:

AllocationMethodAnswersEvaluationsAll 2400 (%)Last 400 (%)
Original budgetLinUCB7200064.04 ± 4.9373.17 ± 4.30
KernelUCB7200062.74 ± 7.0869.58 ± 5.30
NeuralUCB-Diag7200053.46 ± 4.1458.50 ± 5.06
Global Reputation7200057.82 ± 13.9259.75 ± 16.39
Without evaluationHICS7200066.82 ± 2.6875.67 ± 3.55
Added evaluationsLinUCB*7200264070.89 ± 3.0178.83 ± 3.84
KernelUCB*7200264058.19 ± 3.8662.92 ± 3.55
NeuralUCB-Diag*7200264060.42 ± 3.5071.33 ± 4.54
Global Reputation*7200264061.08 ± 13.5663.08 ± 12.76
Added answersLinUCB†9840069.65 ± 3.3778.17 ± 3.41
KernelUCB†9840068.78 ± 6.8173.33 ± 6.76
NeuralUCB-Diag†9840060.21 ± 2.2967.17 ± 4.93
Global Reputation†9840061.92 ± 13.4662.92 ± 14.77
Full HICSHICS7200264073.17 ± 1.2880.92 ± 0.38

Accuracy (%), mean ± sample SD across three configurations. An asterisk (*) marks evaluation-augmented baselines; a dagger (†) marks answer-augmented baselines. All 2400 reports full-stream accuracy; Last 400 reports accuracy on the final 400 tasks.

The same results are in Table 11, Appendix G of the revised manuscript. Accuracy (%), mean ± sample SD over three configurations. An asterisk marks evaluation-augmented baselines; a dagger marks answer-augmented baselines. The evaluation budget comprises 2,400 ordinary and 240 anchor-pair requests. Evaluation-augmented methods retain their quality learners and use the same evaluator-selection, calibration, and weighting protocol. The added-answer group selects four nodes per task and a fifth on 240 predetermined tasks.

At 7,200 requests, HICS without evaluation exceeds the strongest baseline, LinUCB, by 2.78 points overall and 2.50 points in the final window. At 9,840 requests, full HICS exceeds evaluation-augmented LinUCB by 2.28/2.08 points and answer-augmented LinUCB by 3.51/2.75 points. The advantage thus remains when the extra budget is spent on either evaluations or answers. This comparison controls request count; token use, latency, and monetary cost are separate measures. The full results are now in Appendix G.

AuthorsOpenReview ↗

2. Sensitivity to collusive evaluators (Weakness 2, Question 2)

Thank you for raising this concern. We have extended the collusive-evaluator analysis to examine how performance changes with the number of colluding nodes and the identity of the evaluator actually selected. The results are included in Appendix I.

The same colluding set can answer and evaluate. Its members retain correct outputs when successful and otherwise coordinate on a shared wrong answer; as evaluators, they favor that wrong answer and discourage the others. We increase the colluding population from 0 to 48 while keeping node abilities, effort, and potential correctness fixed.

Please see Figure 6 in Appendix I of the revised manuscript. It compares five methods at approximately 8% and 31% GT, with two curves for each method according to whether the selected evaluator is colluding.

Selecting a colluding evaluator is generally associated with lower accuracy, with a clearer separation as the colluding population grows. Performance also tends to decline at larger colluding populations. This deterioration is more pronounced with sparse GT: fewer verified outcomes leave the system more exposed to misleading feedback, whereas higher GT availability helps maintain accuracy. Across the plotted conditions, HICS achieves the highest mean accuracy in most cases, with a particularly consistent lead when a noncolluding evaluator is selected. LinUCB leads in a few of the remaining conditions.

The selection records also show that HICS limits exposure to colluding evaluators: with half the population colluding and sparse GT, only about 5% of its ordinary evaluation requests go to colluders. Together with the accuracy curves, this supports the value of learning evaluator reliability when feedback can be manipulated. The two curves describe outcomes under the system's actual selections and learning histories; evaluator judgments are used to update future decisions.

I appreciate the authors’ detailed rebuttal and substantial additional experiments. These new results partially address my original concerns, yet important limitations still exist. I will keep my rating as weak acceptance.

For the budget comparison. Results in Appendix G rule out that HICS gains purely come from extra evaluation calls. The augmented bandit baselines reuse HICS evaluator pipeline and do not natively model noisy weak feedback. It remains unclear whether a properly adapted bandit method could narrow the performance gap. A clear footnote should be added to main Table 3 to note its unbalanced‑budget setting and direct readers to equal‑budget comparisons in appendix.

For colluding evaluator robustness. The new collusion sweep shows the system can reduce calls to malicious evaluators. All tested adversaries follow fixed scripted behaviour. Adaptive strategic manipulation mentioned in the paper’s motivation is still unexamined. Relevant stress test data stays within appendices. The obvious performance degradation under heavy collusion needs explicit discussion in main limitations.

Thank you for taking the time to read our rebuttal and examine the additional experiments. We sincerely appreciate your careful follow-up and the specific suggestions for improving the paper.

We agree that our augmented bandit baselines retain their original learners while sharing a common evaluation pipeline, and that a dedicated treatment of noisy weak feedback could further improve their performance.

We have added a blue-marked budget note below Table 3, making the unequal budgets explicit and directing readers to Appendix G. We have also added a blue-marked paragraph in the main limitations discussing the degradation under heavy collusion, particularly with sparse GT, and clarifying that our adversaries follow fixed scripted behavior. Adaptive strategic manipulation remains unexamined.

The updated revision incorporates both changes. Thank you again for helping us make the comparison scope and the remaining limitations clearer.

Reviewer_EQdoOpenReview ↗
Rating
2
Confidence
2
Informativeness
1
Presentation
2
Soundness
2
Read review
Paper summary

The paper proposes HICS (Heterogeneous Intelligence Coordination System), which comprises an external routing and quality-control framework that learns task-conditioned execution quality when public descriptions may not reflect nodes’ true reliability. It combines learned task geometry, node-local rolling quality expectations, and a direct contextual estimate, with separate executor and evaluator reliability states for learning from weak feedback. Validation uses a semi-synthetic medical benchmark and controlled simulations, with baseline comparisons and ablation studies examining routing quality under partial feedback and unreliable node behaviour.

Critical strengths
  • Coordinating LLMs and agents, human workers, and human–AI hybrid systems is an interesting and potentially valuable research direction.
  • Comparisons with multiple baseline methods provide evidence for the effectiveness of HICS in the evaluated settings.
Critical weaknesses
  • The manuscript states that nodes may “exert different effort levels” and present “public descriptions that do not match their true reliability,” but provides limited explanation and support for these assumptions. Relevant references or a concrete motivating example would help clarify these assumptions and their practical relevance.
  • The paper emphasizes heterogeneous nodes, including human workers and human–AI hybrid systems, but the medical experiments use prompted configurations of the same GPT-5.5 backend. At a minimum, the evaluation should include different underlying models to better support this broader setting; otherwise, the scope of the claims should be narrowed.
  • The ablations do not demonstrate consistent benefits from anchor calibration and adaptive weighting, as the authors acknowledge. The main text should more clearly explain when these components are beneficial and justify their inclusion in the final framework, particularly given the added complexity.
Questions for authors

please see the weaknesses above

2 comments
AuthorsOpenReview ↗

1. Node construction, effort, and heterogeneity (Weaknesses 1 and 2)

We apologize for the late response, following our recent CVPR submission. We greatly appreciate your thoughtful comments. Your first two concerns are closely related, so we address the motivation and the construction together.

Why descriptions and performance can differ. Two providers may both advertise general medical question answering, while one is stronger on image interpretation and the other on evidence retrieval. Their responses may also depend on how much effort they spend checking an answer. Public descriptions therefore provide an incomplete account of task-specific performance. Related issues of unknown expertise and adversarial labels have been studied in crowdsourcing, for example by Whitehill et al..

How we construct the nodes. In the medical experiments, GPT-5.5 nodes receive prompts assigning different specialties, together with private-profile matching rules that constrain which questions they can answer successfully. They share a general clinical public profile, so execution history reveals differences that the description alone does not. The simulation extends this construction with task-specific ability, variable effort, misleading profiles, and coordinated errors. HICS learns the resulting execution quality from outcomes. The revised Sections 4.1 and 4.2 explain these mechanisms explicitly.

Using a single medical backend lets us examine whether routing learns the imposed specialization differences. Conditioned language models have also been used to construct simulated populations in Argyle et al. and Park et al.. We have not added different backends or a human study; these remain extensions of the current evaluation. Our emphasis here is on producing and measuring differences in task-specific competence, with additional effort variation in simulation.

Do these nodes actually differ? The new analysis in Appendix F measures each node on each benchmark or task family. The heatmaps show distinct strengths: some nodes concentrate on particular areas, others provide moderate performance across several areas, and a few simulated generalists perform relatively well across families. The most suitable node therefore changes with the task. These measurements support the use of the constructed populations to study heterogeneous routing, while human and hybrid nodes remain part of the broader motivation for the framework.

Please see Figure 4 in Appendix F of the revised manuscript, which reports node accuracy across the four medical benchmarks and six simulated task families.

AuthorsOpenReview ↗

2. When anchor calibration and adaptive weighting help (Weakness 3)

Thank you for this suggestion. We have expanded the ablation analysis to examine the feedback conditions under which each component is useful, and added the results to Appendix H.

We compare approximately 8% and 31% GT availability, meaning the fraction of tasks whose correctness is verified and revealed for learning. With honest evaluators, judgments follow the original noisy evaluation rule even when answerers can collude. With collusive evaluators, members of the colluding group can also manipulate judgments to favor their shared wrong answer. We vary the number of colluders from 0 to 24 and use paired comparisons over the same three configurations.

The components address different parts of this process. Anchor calibration uses labeled reference answers to check an evaluator's acceptance and rejection decisions, providing evidence for its reliability estimate. It is therefore especially relevant when evaluator judgments can be manipulated. Adaptive weighting controls how strongly an evaluator's judgment updates executor quality: a more reliable evaluator receives greater influence, while misleading reliability estimates can give that influence to the wrong evaluator.

Anchor calibration gain (pp).

EvaluatorsGT0 colluders6121824
Honest~8%-0.57-0.58-0.53-0.54-0.39
Honest~31%-2.33-2.32-2.32-2.43-2.21
Collusive~8%-0.57-1.53-1.26+2.81+2.85
Collusive~31%-2.33-0.10+2.26+0.72+0.81

Adaptive weighting gain (pp).

EvaluatorsGT0 colluders6121824
Honest~8%+1.04+1.07+1.00+1.00+1.10
Honest~31%-0.08-0.07-0.03-0.31-0.07
Collusive~8%+1.04-1.12-0.35+0.79-1.19
Collusive~31%-0.08+1.62+1.51+1.12+0.71

Values are the mean paired full-stream accuracy differences over three configurations: full HICS minus the corresponding ablation. Positive values favor the component. The anchor ablation retains all requests but discards anchor calibration evidence; the weighting ablation uses fixed weight 0.55. The zero-colluder reference is shared. The same results appear in Figure 5, Appendix H of the revised manuscript.

Anchor calibration. When evaluations follow the honest rule, adding anchors lowers accuracy in these configurations. When evaluators can collude, the gain becomes positive in several stronger-contamination settings: at sparse GT it is clearest with 18–24 colluders, while at higher GT it appears from 12 colluders onward. This pattern is consistent with anchors being most valuable when they supply information needed to identify misleading evaluators. Their effect also depends on how that information changes evaluator selection and feedback weights.

Adaptive weighting. With honest evaluators and sparse GT, weighting improves accuracy by about one point: it can emphasize useful evaluations when direct supervision is limited. With more GT, the extra benefit is small. Under collusive evaluation, the pattern changes. With higher GT, weighting helps at all four nonzero colluder counts, consistent with verified outcomes supporting more informative reliability estimates. With sparse GT, most effects are negative: limited evidence makes it harder to distinguish helpful and misleading evaluators, so weighting can amplify unreliable judgments.

These results explain the earlier ablations. The main experiment uses honest evaluators and approximately 31% GT, a region in which anchors reduce accuracy and adaptive weighting adds little. The broader analysis shows why the two components are included: their value is in controlling weak feedback across different reliability conditions, particularly when evaluations are contaminated and sufficient reference evidence is available. We have updated the discussion to explain these roles and their observed operating conditions.

Reviewer_z3q2OpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper considers the task of routing in a global multi-agent system that comprises of multiple nodes (AI/human/hybrid) that advertise their capabilities. The work introduces HICS - a quality control framework that learns which nodes are reliable and execute the task they promised using available feedback. Experiments demosntrate that HICS does better than alternative baselines like KNN/UCB on a medQA task setup.

Critical strengths
  1. The paper tackles a futuristic problem that might be how the internet evolves - nodes each offering capabilities/small task execution that need to be stitched together.
  2. The ideas and framework seem to be sound.
Critical weaknesses
  1. The writing is not great - it's clear that most of it is AI-generated, but the style and information density make it difficult ot parse what is actually going on. For example, it's hard for me to fully understand the simulation setup in 4.2 despite reading it multiple times.
  2. The experiments also leave several questions open: a) there is no human node tested despite the motivation in abstract. This would be useful to add b) There is no single-agent baseline - I would like to see how well that would do c) Experiments limited to just medical QA and the model is always gpt-5.5 so it's hard to see if this result would hold to more settings.
Questions for authors

See weaknesses above. Would love to get authors' responses on those.

2 comments
AuthorsOpenReview ↗

1. Clarifying the experimental setup (Weakness 1)

We apologize for the late response, following our recent CVPR submission. We greatly appreciate your comments and your encouraging assessment of the problem and framework. Our limited writing experience led to several unclear explanations, and we are sorry for the difficulty this caused. We have revised Section 4.2 and other passages where the setup could be ambiguous. To keep this revision focused on the central issues, we have concentrated on those passages; if given the opportunity, we will further improve the clarity of the manuscript as a whole.

Nodes and task domains. The medical experiments combine four benchmarks covering different clinical question types and image modalities. We use GPT-5.5 with prompts assigning different specialties and a private-profile matching rule: questions below a node's fit threshold receive a controlled incorrect answer, while matched questions use its cached response. This gives nodes different strengths across the task stream. The simulation similarly generates tasks and specialists across six task families, with task-dependent ability and high- or low-effort behavior affecting success.

Feedback and execution. Reference answers determine correctness, but only the outcomes selected by the GT mask are revealed for learning. HICS selects nodes, obtains their answers, and applies the answer aggregation mechanism in Section 3.3. Medical routing is evaluated with one answerer and with three answerers combined by majority vote; simulation uses three answerers with quality- and confidence-weighted voting. Medical peer agreement can supply weak feedback. Simulation additionally selects an evaluator outside the answer set to score candidate answers, and verified outcomes calibrate evaluator reliability. Feedback updates subsequent routing decisions.

Misleading descriptions and collusion. The simulation extends the medical setting with nodes whose attractive public profiles overstate their actual quality. Colluding answerers preserve correct outputs but coordinate on a shared wrong answer when they fail. In the evaluator-collusion analysis, members of the same group can also favor that shared wrong answer when evaluating others. These settings test whether execution history and feedback reliability help the system route despite misleading descriptions and coordinated errors.

AuthorsOpenReview ↗

2. Human nodes, fixed-node baselines, and evaluation scope (Weakness 2)

Thank you for these suggestions. We have added the missing fixed-node comparisons and directly measured the differences among our constructed nodes.

(a) Human nodes and (c) model/domain coverage. We have not added a human-participant experiment because of the recruitment, evaluation workload, and associated cost. The present experiments examine how routing learns from task-dependent differences among nodes; they are not intended to reproduce the full behavior of human participants. Role-conditioned LLM simulation has been explored in Argyle et al. and Park et al.. Our focus is to construct nodes with different task-specific competence through prompts and profile-based rules, and to study additional effort differences in simulation.

To examine these differences, we measured each node's success rate on each benchmark or task family. The heatmaps show clear changes in which nodes perform well across tasks. Some nodes specialize in a particular benchmark or family, others have more even but moderate performance, and the simulation also contains a small number of generalists with relatively strong performance across families. This provides useful variation for task-conditioned routing even when the medical nodes share a backend.

Please see Figure 4 in Appendix F of the revised manuscript, which reports node accuracy across the four medical benchmarks and six simulated task families.

The medical benchmarks provide a relevant setting because their question types and modalities require different expertise. The simulation extends the evaluation to larger pools with variable effort, misleading profiles, and coordinated behavior. We acknowledge that different underlying models and other real application domains remain to be evaluated, alongside human participation.

(b) Fixed-node baseline. We evaluated every node on the original main-experiment workload and selected the strongest fixed node after evaluation. The results have been added to Tables 1 and 3:

SettingBest fixed nodeHICS
Medical, 100% GT65.75 ± 0.0075.46 ± 0.63
Medical, 50% GT65.75 ± 0.0071.53 ± 2.28
Medical, 10% GT65.75 ± 0.0066.03 ± 1.15
Simulation, main setting48.79 ± 16.5073.17 ± 1.28

Accuracy (%), mean ± sample SD. Medical HICS uses five algorithm seeds; the deterministic fixed policy has one cached score independent of the seed. Simulation uses three configurations, with the best fixed node chosen separately in each. Medical policies both use one answer per task. In simulation the fixed policy uses one answer, while full HICS uses three answers and additional evaluations; Appendix G reports request-matched comparisons.

The results show the value of changing node selection across the diverse task stream, particularly with more verified feedback. At 10% medical GT the mean improvement over the best fixed node is small, at 0.28 percentage points.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Summary of Revisions

We sincerely thank all reviewers for their constructive feedback and the Area Chair for their time and coordination. Each reviewer’s comments have helped strengthen the paper. We apologize for responding late, following our recent CVPR submission. Our limited writing experience led to unclear experimental descriptions. We have rewritten the core setup and addressed the main ambiguities, focusing this revision on the substantive concerns raised. If given the opportunity, we will further improve the manuscript’s clarity.

We completed additional analyses and revised the manuscript in five areas.

1. Experimental setup and node heterogeneity (Sections 4.1–4.2; Appendix F, Figure 4).

We clarified how prompts and private-profile matching rules create medical nodes with different specialties, and how simulation adds variable effort, misleading profiles, coordinated errors, and independent evaluators. We also explained answer aggregation, feedback sources, and update timing. Figure 4 measures node accuracy across benchmarks and task families, showing specialists, nodes with more even performance, and a few simulated generalists. Using a single LLM backend therefore does not make the nodes behaviorally homogeneous or prevent a meaningful evaluation of heterogeneous routing: prompts and profile-based rules produce distinct task-dependent capabilities. The revised description and analysis clarify this construction (z3q2 W1–W2; EQdo W1–W2).

2. Fixed-node baselines (Section 4.1, Table 1; Section 4.2, Table 3).

We evaluated every fixed node on the original workloads and added the strongest fixed-node reference to both main tables (z3q2 W2). In the one-answer medical setting, the best fixed node achieves 65.75% accuracy, compared with 75.46%, 71.53%, and 66.03% for HICS under full, half, and sparse GT. The simulation table includes the strongest fixed node selected separately for each configuration, with its one-answer budget stated explicitly.

3. Matched interaction budgets (Section 4.4; Appendix G, Table 11).

To address HICS’s additional evaluation requests (qbdK W1/Q1), we compared HICS without evaluation, four original baselines, and baseline variants spending the additional budget on evaluations or answerers. At 9,840 total requests, full HICS achieves 73.17% full-stream accuracy, compared with 70.89% for evaluation-augmented LinUCB and 69.65% for answer-augmented LinUCB. A new note below Table 3 makes the original budget difference explicit and points to these comparisons.

4. Anchor calibration and adaptive weighting (Appendix H, Figure 5).

We expanded the component analysis across GT availability, colluding populations, and honest or collusive evaluator behavior (EQdo W3). The results explain the limited gains in the original main setting, which uses honest evaluators and relatively more verified feedback. In the broader analysis, anchor calibration helps in several contaminated-feedback settings, while adaptive weighting is useful when reliability estimates distinguish informative from misleading evaluations. We revised the discussion to explain both components’ roles and operating conditions.

5. Collusive evaluator sensitivity and limitations (Appendix I, Figure 6; Section 5).

We extended the colluding population from 0 to 48 nodes and analyzed accuracy by the selected evaluator’s identity (qbdK W2/Q2). Accuracy generally declines as collusion grows, especially with sparse GT; HICS has the highest mean accuracy in most plotted conditions. With half the population colluding and sparse GT, only about 5% of HICS’s ordinary evaluation requests go to colluders. Following the reviewer’s further suggestion, the main limitations now explicitly discuss degradation under heavy collusion and the use of fixed scripted attackers.

All additions and revised passages are marked in blue. We thank every reviewer for their careful assessment and the Area Chair for overseeing the discussion. Their feedback has improved both the evidence and presentation. We welcome further questions.

Best regards,
Authors of Submission 41262

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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