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Under review as a conference paper at ICLR 2027

Quotient-First Decoding: Sharp Truncation Gaps Without Support Loss

Abstract

Can a truncation decoder change its output law when only the representation of probability mass changes? We analyze exact mass-preserving refinements relative to a supplied outcome quotient. We characterize exactly the outcome laws reachable by nucleus sampling without changing its support. At each fixed parent law, the fine-uniform-refinement limit simultaneously maximizes every convex f-divergence from the reference decoder. The sharp one-step total-variation (TV) supremum is ; its horizon- counterpart is . We identify the mechanism under threshold-prefix compatibility: refinement thins the boundary outcome, preserves the conditional law above it, and can strictly sharpen the distribution. A binary likelihood-ratio factorization explains how this distortion propagates along autoregressive paths. Quotient-first decoding removes it by aggregating before truncation; classical conditional-preserving projection characterizes its unique faithful lift. In state-preserving experiments on three real language models and 120 held-out ARC-Challenge, GSM8K, and MMLU prompt families, Qwen3-8B reaches path TV (95% confidence interval (CI) [0.176, 0.195]). Uniform refinement reaches 0.256 ([0.245, 0.267]) with identical path support. An exact, locally canonical byte quotient gives ; quotient-first replay agrees with the reference kernel to . These results explain representation dependence and establish an exact, conditional-faithful remedy for the supplied outcome quotient.

Primary area:
learning theory
Keywords:
language model decoding, nucleus sampling, truncation sampling, representation coherence, quotient-first decoding, representation refinement, total variation distance, autoregressive generation

Reviews

Among:
Shape:
1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 4 reviews, above 27% of the others.
Reviewer_6H3VOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
1
Soundness
3
Read review
Paper summary

I'll try to explain the article by explaining what I understand as the most natural real world application. The article is a theoretical one which mentions these applications in passing.

Suppose we have some ML model working on tokens, and we wish to group some tokens together into a cluster of similar tokens in terms of what kind of outcome they produce. We might think of image models giving two patches of pixels which are nearly identical, or similar problems for audio codebooks. Since not every possible patch of pixels makes it into the codebook, we have problems where some patches of pixels have many tokens which could reasonably faithfully represent them, whereas other patches of pixels are only well represented by one token. In particular, a cluster of total model probability p may be represented by a single token of probability p or by many tokens of probability p/n. This property interacts very badly with truncation sampling (such as top-p), where tokens are kept or discarded based on their individual probability, not the probability of the cluster to which they belong.

This problem has been noted, and a potential fix suggested, in prior work. The present work is concerned with theoretical bounds on how bad the phenomenon can be of distorting the mass of sequences of clusters of tokens, even in the case that the sequence of clusters of tokens survives truncation.

Critical strengths

The theory is well explained and the experiments are competently done, I have no issues at all with the proofs/ experimental execution.

Critical weaknesses

I am used to reading both mathematics and machine learning, and so should be in the target audience for this paper, but I find the first two pages almost impenetrable. I did not understand from the abstract or first page that, on a basic level, this article is about splitting the mass of one token into many subtokens, and how this distorts probability mass.

Furthermore, I don't get from reading the article a sense of how practically important the work is. This is, I think, largely a choice of the authors to present their work as being about abstract clusterings of tokens, rather than about a specific type of model. But this presentation assumes that the reader is already familiar with how the basic question affects real world models and is convinced that this question needs solving.

I think I find the two example experiments rather artificial, particularly the first experiment which looks at taking a language model and randomly splitting each token into eight alternative tokens with the same total mass as the original token but the proportion in each alternative token being randomly assigned. I am perfectly convinced that this procedure interacts badly with top-p sampling, but not really convinced that this is a problem.

Questions for authors

I'm afraid I don't really have any questions about your work that would cause me to increase my score. I think there is very substantial value in purely theoretical work, and artificial experiments can be of value, I think some version of your work could be useful. But for a general audience conference like ICLR I think you need to do a lot more to explain (gently) to your reader the problem you are solving and how large it really is.

4 comments
AuthorsOpenReview ↗

The closing explanation request: Splitting before abstraction

Weakness 1: the first pages do not explain the basic operation. Thank you for your constructive feedback. We agree that the opening introduced abstraction before explaining mass splitting. To address this, we have rewritten the abstract and added a short numerical example as the first paragraph of the introduction, before quotient notation. Both are on p. 1.

Weakness 1, the example now used in the opening. We appreciate your request for a direct explanation. Suppose three outcomes have probabilities (0.6,0.3,0.1)(0.6,0.3,0.1) and the nucleus threshold is 0.80.8. Truncating outcomes directly keeps the first two and gives (2/3,1/3,0)(2/3,1/3,0). Now give each outcome three equal-probability labels. Label-level truncation keeps all three labels of the first outcome but only two of the second. After merging labels, the law is (3/4,1/4,0)(3/4,1/4,0). The first outcome's probability rises from 66.7% to 75%, an 8.3-percentage-point change, although the same two outcomes remain possible.

Your closing request to explain gently what the analysis contributes. Thank you for asking us to connect the example to its purpose. We have added a practical-design paragraph in Section 4 (p. 6): compare the retained fractions to test invariance, then compute the largest possible same-support distortion from the original nucleus. Theorem 3.1 determines every attainable same-support law and its exact largest error, so the analysis replaces an isolated example with a complete sensitivity calculation. When the application requires preservation, aggregating before truncation enforces its chosen outcome law.

Your closing request for an accessible presentation of the mechanism. We appreciate the distinction between sound mathematics and an accessible introduction. We have also moved the existing uniform-refinement illustration beside its finite-multiplicity result, now Figure 2 (p. 5). It shows how the boundary outcome is retained only in part and how the finite-refinement error approaches the sharp bound. This is an explanatory relocation of an existing analytic figure, not a new experiment. The rewritten abstract, new opening example, relocated illustration, and explicit design paragraph answer your presentation concern while preserving the technical development. Our second comment addresses Weaknesses 2 and 3 in their original order.

AuthorsOpenReview ↗

Practical scale and the purpose of the controlled intervention

Weakness 2: how practically important and how large is the effect? Thank you for asking us to distinguish mathematical possibility from natural scale. We added a terminal-action evaluation: legal one-token answer renderings are mapped to the same selected option, and generation stops. It covers all 1,172 ARC-Challenge and 14,042 MMLU questions separately for Qwen3-8B, Qwen2.5-0.5B-Instruct, and OLMo-3-7B-Instruct, at temperature 0.7 and top-p 0.9. Across six cells, mean one-step TV ranges from 5.7×10−55.7\times10^{-5} to 1.3×10−31.3\times10^{-3}. Fewer than 1.63% of questions per cell change support and contribute over 99.99% of each mean; same-support means are below 4.6×10−94.6\times10^{-9}. Section 5.4 (p. 9) and Table 3 (p. 10) report the scale, settings, and support decomposition.

This is a useful practical result: it identifies a concrete natural terminal-action setting with low observed representation sensitivity, while the controlled experiment separately shows that large same-support sensitivity is possible. The result therefore resolves the scale question without conflating typical natural magnitude with worst-case theory. Your image/audio analogy motivates grouping, but approximate similarity alone does not establish identical continuation states.

Weakness 3: why use an artificial random split? Thank you for separating a controlled mechanism test from evidence of prevalence. Its purpose is to hold the model, tokenizer, and untruncated kernel fixed at each shared history, isolating decoder order. Random split imbalance is unnecessary: deterministic uniform eight-way splitting gives mean parent-path TV 0.256 [0.245, 0.267] at 64 tokens over 120 Qwen3-8B families, with support preserved in exact arithmetic and zero recorded one-sided contribution. This experiment was already in the submission; Figure 3 (p. 7) retains its result. The additional natural-action and task studies answer different practical questions rather than relabeling this controlled result as new evidence.

Weakness 2, direct task consequences. We appreciate your practical-impact concern and added the full-task evaluation also requested by 9EtP.

PolicyARC-Challenge accuracyGSM8K accuracy
Parent-first top-p40.27%37.00%
Quotient-first40.27%37.00%
Uniform refinement40.78%38.21%
Dirichlet refinement40.36%37.68%
Greedy43.43%43.29%

The refinement point estimates are slightly higher than parent-first on both tasks. Uniform-minus-parent is +0.51 percentage points on ARC [−0.26, 1.37] and +1.21 on GSM8K [−0.83, 3.26]; neither refinement differs significantly from parent-first after Holm adjustment under the single-seed paired protocol. Thus the experiment directly measures correctness and does not reveal a distinguishable accuracy penalty or gain, rather than interpreting path separation as an accuracy effect. Section 5.3 and Table 2 (p. 9) report these results. Together with the opening changes, these additions address your request for a clear explanation of the problem and its measured scale. We would be grateful for reconsideration of that clarified contribution. Thanks.

Many thanks to the authors for their work. I don't think the new results on task consequences support the case for viewing Quotient first decoding as an important real world solution. I don't think they work against it either, I'm not quite convinced it's the right experiment. Nevertheless, my conclusion remains substantially unchanged from my original review, I repeat my conclusion from before below -

I'm afraid I don't really have any questions about your work that would cause me to increase my score. I think there is very substantial value in purely theoretical work, and artificial experiments can be of value, I think some version of your work could be useful. But for a general audience conference like ICLR I think you need to do a lot more to explain (gently) to your reader the problem you are solving and how large it really is.

I would add that, while this is opinion, you haven't convinced me of the true utility of this work.

Additional measurements of repeated decoding, and the problem and usefulness they help clarify

Thank you for your thoughtful follow-up. The additional three-model study beyond our first two replies directly measures how sensitivity changes when the operation is applied once or repeatedly throughout generation. These controlled measurements make the design implications more concrete, alongside the natural-interface results discussed below. We included the task-accuracy evaluation requested by 9EtP because we thought it might connect the distributional analysis to practical consequences. Your follow-up helps us focus on the problem the theory addresses and the decisions it helps a decoder designer make.

1. The problem in plain language. Consider an application in which several accepted labels select the same terminal action. Their combined probability is the model's probability for that action. Dividing the same mass among more labels changes its representation but not the underlying action probability. Nevertheless, top-p applied to individual labels can change how often the action is selected. If the application specifies top-p on actions, the implementations can disagree even when they permit exactly the same actions. The terminal setting makes the grouping exact without assuming equivalent future model states for different tokens.

The revised opening illustrates this with probabilities (0.6,0.3,0.1)(0.6,0.3,0.1) and threshold 0.80.8. Direct truncation gives retained action probabilities (2/3,1/3)(2/3,1/3); three equal labels per action change them to (3/4,1/4)(3/4,1/4). The first action becomes 8.3 percentage points more likely. Theorem 3.1 proves that 1/121/12 is the exact largest same-support TV discrepancy for those original masses.

2. What the new controlled experiment adds about magnitude. We varied the frequency of the representation-sensitive operation using uniform eight-way refinement, temperature 0.7, top-p 0.9, 60 fixed prompt families per model (20 each from ARC-Challenge, GSM8K, and MMLU), four generation seeds, and both sampling lanes. Mean parent-path TV at 64 tokens is:

ModelFirst step onlyEvery fourth stepAfter step 32Every step
Qwen3-8B0.00950.1020.1520.249
Qwen2.5-0.5B-Instruct0.03780.1290.1540.265
Olmo 3 7B Instruct0.01550.1280.1700.289

In all twelve settings, the measured discrepancy comes from reweighting shared paths; the recorded one-sided-support contribution is zero. For Qwen3, the first-step-only and every-step 95% intervals are [0.0049, 0.0148] and [0.230, 0.269]. Appendix J.1 and Table 14 report the study. The result shows that initial sensitivity can substantially understate the effect of repeated decoder decisions. Model weights and the untruncated kernel at shared histories remain fixed. This controlled comparison measures the effect under each complete schedule. It shows why assessing the full sequence gives a more informative picture of sensitivity than checking the first decision alone.

For comparison, the earlier natural-scale evidence remains separately identified. The terminal-answer study covers all 1,172 ARC-Challenge and 14,042 MMLU questions for each of the same three models, at temperature 0.7 and top-p 0.9. Conditional on legal answer tokens, mean one-step TV is 0.000057–0.0013. Rare support-changing questions contribute over 99.99% of each mean; same-support means are below 4.6×10−94.6\times10^{-9}. This identifies a natural interface with low sensitivity. Section 5.4 and Table 3 report the finding. One-step action TV and 64-token path TV concern different outcomes and horizons.

3. What useful capability the theory provides. Proposition 2.1 tests whether an implementation preserves the specified outcome policy through its retained fractions. Theorem 3.1 characterizes every attainable same-support law at the original distribution and its exact largest discrepancy. A designer can certify a tolerance without searching through label encodings. When the actual implementation needs correction, aggregation before truncation supplies an exact correction. Section 4 makes these decisions explicit. Together, the theory and new study show how to check a decoder, assess its possible error, and correct it when needed.

Thank you again for reviewing our work. We hope the explanation and additional measurements clarify the problem, its measured scale, and the verification capability provided by the theory. We would appreciate it if you could revisit our responses and reconsider your evaluation in light of the clarified contribution and new evidence. We appreciate your consideration.

Reviewer_vvMoOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

The paper studies how nucleus sampling changes when each token's probability is split among virtual children emitting the same token. It characterizes exactly the outcome laws reachable without changing support, gives sharp one-step and horizon-HH TV gaps, explains them by boundary thinning, and proposes aggregating to the supplied quotient before truncating.

Critical strengths

The results are exact and correct, including the reachability and extremality proofs and both sharpness constructions. The paper separates support preservation from distribution preservation and credits classical results. Experiments hold model state fixed so only decoder order varies, include full-sampling and quotient-first controls, and openly report the small Top-K and byte effects.

Critical weaknesses
  1. Practical significance is not shown. The large effects (D64=0.185D_{64} = 0.185-0.2560.256) come from a constructed intervention, virtual splits. In the one natural quotient studied, token to byte, the effect is small (D32=0.038D_{32} = 0.038) and mostly due to support changes; common-support reweighting, the mechanism the theory analyzes, contributes 0.015 (Table 6). Please identify a practical setting where support-preserving refinement arises and is large.

  2. Novelty is narrow. Aggregate-decode-condition sampling already appears in cluster truncation, the token-versus-byte truncation contrast in Hayase et al., and Prop. 4.1 and B.3 are classical. The new results are correct but short and elementary; the paper should explain what they change for decoder design or analysis.

Questions for authors

What is the byte sampler's order of canonical filtering, temperature, normalization, and truncation inside unfinished tokens?

4 comments
AuthorsOpenReview ↗

Natural magnitude and the analytical contribution

Weakness 1: identify a practical, large support-preserving effect. Thank you for distinguishing controlled sensitivity from natural prevalence. To answer the application question, we added a concrete terminal-action evaluation: legal one-token renderings are mapped to the same selected answer, and generation stops. This supplies a valid outcome grouping without assuming equivalent future model states. The study identifies a low-sensitivity natural setting; it does not establish a large natural same-support effect.

Weakness 1, measured scale and support decomposition. We appreciate your request for magnitude rather than another constructed example. The new study covers all 1,172 ARC-Challenge and 14,042 MMLU questions for each of Qwen3-8B, Qwen2.5-0.5B-Instruct, and OLMo-3-7B-Instruct at T=0.7T=0.7, top-p 0.9. Across six cells, mean one-step TV ranges from 5.7×10−55.7\times10^{-5} to 1.3×10−31.3\times10^{-3}, conditional on legal answer tokens. Fewer than 1.63% of questions per cell change support and account for over 99.99% of each mean; same-support means are below 4.6×10−94.6\times10^{-9}. Section 5.4 (p. 9) and Table 3 (p. 10) state the decomposition and operating point.

This is a useful audit outcome: the framework identifies a concrete natural terminal-action setting with low observed sensitivity. The byte result remains 0.038, with 0.023 one-sided and 0.015 common-support contributions. The complementary large same-support result is the controlled uniform intervention, TV 0.256 [0.245, 0.267] over 120 Qwen3 families. We therefore separate low natural sensitivity at this operating point from the demonstrated possibility of large controlled same-support sensitivity.

Weakness 1, direct task consequences. Thank you for raising practical significance. The additional full ARC/GSM8K Qwen2.5-0.5B-Instruct evaluation, also requested by 9EtP, gives:

PolicyARC-Challenge accuracyGSM8K accuracy
Parent-first top-p40.27%37.00%
Quotient-first40.27%37.00%
Uniform refinement40.78%38.21%
Dirichlet refinement40.36%37.68%
Greedy43.43%43.29%

Both refinements have slightly higher point estimates than parent-first on both tasks. Uniform-minus-parent differences are +0.51 percentage points on ARC [−0.26, 1.37] and +1.21 on GSM8K [−0.83, 3.26]; neither refinement differs significantly after Holm adjustment under the single-seed paired protocol. Thus the study directly measures downstream correctness without presenting the large controlled path-TV result as an accuracy gain. Section 5.3 and Table 2 (p. 9) report the comparison.

Weakness 2: what changes for design or analysis beyond established work? We agree with your attribution and appreciate the request for an operational consequence. Cluster truncation already uses aggregate–decode–condition sampling, Hayase et al. compare token and byte truncation, and the projection and universal-coherence foundations are classical. The new result is the complete fixed-law reachable set, finite realization, common extremizer for every convex f-divergence, and sharp support-constrained limits. The fixed-law bound either certifies that every admissible same-support refinement meets a tolerance or identifies a sharp attainable counterexample; the retained-fraction test determines exact invariance. Section 4 (p. 6) makes these design consequences explicit. Small empirical discrepancies alone are not a certificate. We would appreciate reassessment of these analytical contributions and their practical use.

AuthorsOpenReview ↗

Filtering, temperature, normalization, and truncation inside unfinished tokens

Your question about canonical filtering. Thank you for requesting the precise unfinished-token specification. Candidate leaves are prefix-compatible; the optional additional canonical leaf filter is not applied. Completed-token branches retain the sampler's adjacency-compatibility checks. Consequently, neither branch first canonically filters and renormalizes an unfinished-token subset before applying top-p to that subset.

Your question about the operation order, token-first branch. We appreciate the need to specify exactly where truncation occurs. At each queried token context, temperature is applied to token logits, then token-level top-p is applied and the retained probabilities are renormalized. Those scores enter the prefix-compatible tree aggregation, producing 256 next-byte outcomes plus a shared stop. The resulting byte scores are normalized. No byte-level top-p is applied in this branch. In sequence: temperature, token truncation and normalization, tree aggregation, byte normalization.

Your question about the operation order, byte-first branch. Thank you for asking for the corresponding comparison, it helped the paper. Temperature is again applied to token logits, but token-level truncation is omitted. The same prefix-compatible aggregation produces the byte scores; they are normalized, then byte-level top-p is applied and renormalized. In sequence: temperature, tree aggregation, byte normalization, byte truncation and normalization. The purpose of separating these pipelines is to show that truncation is placed before versus after aggregation, not to imply two different canonical-filtering rules. Both likelihoods are evaluated at the same byte prefix, and the shared stop is absorbing.

The clarification made to answer this question. We acknowledge that the process description must match the implementation. Section 5.2 (pp. 8–9) now describes the prefix-compatible transition law, disabled additional unfinished-leaf filter, and truncation order; Appendix E (p. 25) states the same scope. The supplement retains the exact settings. This is a clarification of the measured byte process, not a new byte experiment or a claim of unrestricted token marginalization. It resolves the operation-order question while preserving the measured values. The finite-law theorems and separate uniform-refinement construction do not depend on this byte implementation.

Thank you.

New evidence for decoder analysis, with the natural-effect and implementation questions kept explicit

Thank you for your careful review. The additional three-model study, beyond the results in our first two replies, directly addresses your second concern: what the analysis changes for decoder design. We keep this design evidence separate from your request for a large natural same-support effect, and we also restate the byte-sampling specification precisely.

1. Your request for a natural, substantial same-support effect. The earlier terminal-action study evaluates legal one-token renderings that select the same answer and terminate generation. It covers all 1,172 ARC-Challenge and 14,042 MMLU questions per model, at temperature 0.7 and top-p 0.9, conditional on legal answer tokens. Across Qwen3-8B, Qwen2.5-0.5B-Instruct, and Olmo 3 7B Instruct, mean one-step TV is 0.000057–0.0013. Fewer than 1.63% of questions per cell change support and contribute over 99.99% of each mean; same-support means are below 4.6×10−94.6\times10^{-9}. These results identify a natural setting with low sensitivity rather than the large natural same-support effect you requested. Section 5.4 and Table 3 state this scope.

2. New experiment addressing your decoder-design concern. We varied the frequency of the representation-sensitive operation using uniform eight-way refinement, temperature 0.7, top-p 0.9, 60 fixed prompt families per model (20 each from ARC-Challenge, GSM8K, and MMLU), four generation seeds, and both sampling lanes. Mean parent-path TV at 64 tokens is:

ModelFirst step onlyEvery fourth stepAfter step 32Every step
Qwen3-8B0.00950.1020.1520.249
Qwen2.5-0.5B-Instruct0.03780.1290.1540.265
Olmo 3 7B Instruct0.01550.1280.1700.289

In all twelve settings, the measured discrepancy comes from reweighting shared paths; the recorded one-sided-support contribution is zero. For Qwen3, the first-step-only and every-step 95% intervals are [0.0049, 0.0148] and [0.230, 0.269]. Appendix J.1 and Table 14 report this additional comparison. The result shows why an initial-step diagnostic can understate sensitivity when the operation is applied repeatedly. This controlled comparison describes complete schedules. Alongside the local diagnostic, it gives designers a reason to check sensitivity across the full sequence.

The practical decision is whether an implementation preserves the specified outcome law and what error it can guarantee. Proposition 2.1 tests the actual encoding through retained fractions. Theorem 3.1 gives the exact largest TV error over admissible same-support refinements,

Sk−1(Sk−ρ)ρSk,\frac{S_{k-1}(S_k-\rho)}{\rho S_k},

where ρ\rho is the nucleus threshold, kk is the retained-outcome count, and SjS_j is the cumulative mass of the first jj ranked outcomes. If this maximum meets the application's tolerance, every such refinement does; otherwise, a violating refinement exists, while the actual encoding is checked separately. Section 4 connects these tests to implementation choices. We credit the established aggregate-first remedy and classical projection foundations; the complete reachable-law characterization, finite realization, common convex-divergence extremizer, and sharp support-constrained limits are the analytical contribution.

3. Your question about unfinished tokens and operation order. Both branches use prefix-compatible candidates. The optional additional canonical leaf filter is disabled, while completed-token branches retain adjacency-compatibility checks. Neither branch first canonically filters and renormalizes an unfinished-token subset before applying top-p.

Token-first: Apply temperature to token logits, then token-level top-p and renormalization, followed by tree aggregation into 256 next-byte outcomes plus a shared stop, and finally byte normalization. There is no byte-level top-p.

Byte-first: Apply temperature to token logits, omit token truncation, perform the same tree aggregation and byte normalization, and then apply byte-level top-p and renormalize. Both likelihoods use the same byte prefix, and the stop is absorbing.

Section 5.2 and Appendix E specify the order and scope. The Qwen2.5 mean 32-byte TV remains 0.038 [0.027, 0.049], including 0.023 one-sided and 0.015 common-support contributions. This is the earlier prefix-compatible byte process, not a new byte experiment or unrestricted token marginalization.

A further answer to your decoder-design concern: a tested attenuation option

Your second concern asks what the analysis changes for decoder design. Alongside the exact diagnostic, the additional attenuation panel provides a concrete option when an outcome grouping is unavailable.

How the mixture works. At each step, use the untruncated distribution with probability 0.25 and top-p with probability 0.75. Implementing this rule requires no grouping of equivalent outcomes. The mixture defines its own sampling policy; the two TV columns below measure the sensitivity of their respective policies.

Matched results across three models. We tested the 25% mixture on 30 fixed prompt families, ten each from ARC-Challenge, GSM8K, and MMLU, with two generation seeds, both sampling lanes, uniform and Dirichlet eight-way refinement, temperature 0.7, top-p 0.9, and a 128-token horizon. The table reports mean parent-path TV; the paired change is mixture minus top-p:

ModelRefinementTop-p TVMixture TVPaired change [95% CI]
Qwen3-8BDirichlet0.3800.251−0.129 [−0.204, −0.055]
Qwen3-8BUniform0.4090.271−0.138 [−0.192, −0.083]
Qwen2.5-0.5B-InstructDirichlet0.4560.278−0.178 [−0.247, −0.107]
Qwen2.5-0.5B-InstructUniform0.4200.289−0.132 [−0.182, −0.079]
Olmo 3 7B InstructDirichlet0.3610.243−0.118 [−0.178, −0.059]
Olmo 3 7B InstructUniform0.4600.347−0.113 [−0.159, −0.066]

All six reductions survive Holm adjustment over 24 endpoint contrasts, covering four nonzero mixture weights in each model/refinement cell. The nominal paired 95% intervals use 20,000 task-stratified family-bootstrap resamples. Seeds and lanes are averaged within each family, and the three tasks receive equal weight. Appendix J.2 and Table 15 report this comparison.

Equation (23) in Section 5.4 gives the exact attenuation of the one-step gap; the table measures path sensitivity over a 128-token horizon. Together with the local diagnostic, this provides a concrete design choice: exact preservation through quotient-first decoding when a grouping is supplied, or a full-sampling mixture to reduce sensitivity when it is unavailable. The consistent reductions across all six tested settings make this an experimentally supported option for decoder design.

Thank you again for reviewing our work. We hope these clarifications and the additional design evidence address your questions, and we would appreciate it if you could revisit our responses and reconsider your evaluation in light of the contribution and evidence provided. We appreciate your consideration.

Reviewer_9EtPOpenReview ↗
Rating
2(−2)
Confidence
2
Informativeness
3
Presentation
3
Soundness
3
Read review
Paper summary

This paper reveals a counterintuitive flaw in truncation decoders (particularly nucleus sampling in large language models): even when the candidate outcome support remains entirely unchanged, merely altering the granularity of probability mass representation triggers a "boundary thinning" mechanism—where the truncation threshold cuts inside the boundary outcome, thinning its retained fraction while higher-ranked outcomes are boosted via renormalization, thereby strictly sharpening the sampling distribution and accumulating measure drift along the autoregressive path.

To address this issue, the paper proposes "quotient-first decoding"—a method that aggregates probability mass onto the quotient space prior to truncation and subsequently lifts it back using the reference conditional distribution, completely eliminating representation distortion.

The experimental on real language models results demonstrate that under 100% identical path support, the path total-variation (TV) distance reaches up to 0.256, while quotient-first replay successfully recovers the reference kernel to floating-point precision.

Critical strengths
  1. Uncovering the microscopic mechanism of 'boundary thinning': refinement makes the truncation cutoff fall inside the same parent outcome, thinning its probability and inducing majorization on the resulting decoded distribution.
  2. The paper features rigorous theoretical derivations and very clear, informative figures that effectively convey complex probabilistic concept.
Critical weaknesses

Absence of downstream task performance metrics: It remains unclear to engineering-minded readers whether the reported path-level drift D_64=0.185 actually benefits, degrades, or is inconsequential to real-world task accuracy and generation quality.

Questions for authors
  1. On benchmarks such as GSM8K or ARC-Challenge, does this boundary-thinning-induced sharpening increase greedy tendencies and hurt diversity, or could it actually benefit reasoning accuracy? Could the authors provide any qualitative or preliminary observations on downstream impact?
  2. Can smoothing the hard truncation step effectively curb the cumulative drift from boundary thinning without needing to explicitly define a quotient mapping?
4 comments
AuthorsOpenReview ↗

Accuracy, greediness, and diversity

Downstream-performance weakness and Question 1: does sharpening help or hurt accuracy? Thank you for requesting downstream evidence. To address your comment, we added complete evaluations on both benchmarks you suggested, ARC-Challenge and GSM8K. The result is reassuring but deliberately scoped: both refinements have slightly positive accuracy point estimates on both tasks, while the paired analysis does not establish a statistically distinguishable benefit or harm. This is not an equivalence claim; the evaluation directly connects the distributional analysis to answer correctness.

Question 1, the complete experimental comparison. We appreciate your request for benchmark observations. All policies use Qwen2.5-0.5B-Instruct, identical prompts and budgets, and all 1,172 ARC and 1,319 GSM8K questions. Stochastic policies use T=0.7T=0.7, top-p 0.9, and seed 101; greedy uses seed 0. Refinements have multiplicity eight, with Dirichlet split seed 11. Accuracy percentages and correct-answer counts are:

PolicyARC-Challenge, n=1,172GSM8K, n=1,319
Parent-first top-p40.27 (472)37.00 (488)
Quotient-first40.27 (472)37.00 (488)
Uniform refinement40.78 (478)38.21 (504)
Dirichlet refinement40.36 (473)37.68 (497)
Greedy43.43 (509)43.29 (571)

Main finding. Quotient-first exactly matches parent-first in this coupled implementation, while both refinement policies have slightly higher point estimates on both tasks. The paired analysis below does not establish a distinguishable refinement-related gain or loss.

Question 1, comparison conditions and uncertainty. Thank you for asking whether the change helps or hurts, rather than only whether distributions differ. ARC has an eight-token direct-answer cap; GSM8K has a 512-token reasoning cap. Capped and unparsable outputs stay in the denominator. Scoring uses the last standalone legal ARC label and the final marked GSM8K number or declared last-number fallback. Uniform-minus-parent differences are +0.51 percentage points [−0.26, 1.37] and +1.21 [−0.83, 3.26]. Neither uniform nor Dirichlet differs significantly from parent-first after Holm adjustment over all ten policy pairs on each of two datasets. Greedy is higher on GSM8K: +6.29 points [3.56, 9.02], with bootstrap-based Holm-adjusted p≈0.001p\approx0.001. The 20,000-resample question-bootstrap intervals condition on the checkpoint and stochastic seed, not between-seed variability. Section 5.3 and Table 2 (p. 9) give the accuracies; Appendix H (p. 26) now also states the greedy contrast.

Question 1, greediness and diversity. We acknowledge your concern that sharpening could affect diversity. Local concentration is not greedy decoding: under threshold-prefix compatibility, thinning boosts interior probabilities while preserving their ratios, and the refinement policies remain stochastic. The theorem concerns local entropy, not path entropy or semantic diversity, which was not measured. All 2,491 coupled parent/quotient-first pairs match in saved tokens, text, and termination flags as an implementation check; exact coherence follows from the construction. The accuracy results therefore answer the task question without substituting accuracy for diversity or finite path agreement for a theorem.

AuthorsOpenReview ↗

Reducing cumulative drift without an explicit quotient

Question 2, attenuation without a grouping. Thanks for your comment on curbing drift without defining a quotient. We added an exact attenuation argument and a matched real-model evaluation. Both support an affirmative answer for attenuation, while distinguishing it from exact representation invariance.

Question 2, the mathematical mechanism. We appreciate your suggestion to modify hard truncation. Mix the decoder with full sampling, Dϵ=(1−ϵ)D+ϵId⁡D_\epsilon=(1-\epsilon)D+\epsilon\operatorname{Id}. At a shared history, mass preservation adds the same ϵp\epsilon p component to both orders, giving

TV⁡(Pϵ,Qϵ)=(1−ϵ)TV⁡(P,Q).\operatorname{TV}(P_\epsilon,Q_\epsilon)=(1-\epsilon)\operatorname{TV}(P,Q).

With original conditional gaps bounded by δt\delta_t over shared histories, coupling gives

TV⁡(PHϵ,QHϵ)≤1−∏t=1H[1−(1−ϵ)δt].\operatorname{TV}(P_H^\epsilon,Q_H^\epsilon)\le1-\prod_{t=1}^H[1-(1-\epsilon)\delta_t].

This bounds accumulation without an explicit grouping; it does not predict linear scaling of measured path TV.

Question 2, the additional matched evaluation. Thank you for asking whether this can curb cumulative drift in practice. We evaluated non-thinking Qwen3-8B on 60 families, 20 each from ARC, GSM8K, and MMLU, with T=0.7T=0.7, eight-way Dirichlet refinement, split seed 11, and generation seeds 101 and 211. Each arm has 240 dual-scored paths through 64 tokens. Means average seeds and lanes within family; matched family differences are resampled within task with equal task weighting.

DecoderMean parent-path TVResult relative to top-p
Top-p(0.9)0.218Reference
25% full-sampling mixture0.156−0.0618 [−0.0897, −0.0351]
Power decoder, exponent 1.250.0381 [0.0335, 0.0429]Separate smooth decoding target

The matched mixture result is positive and statistically resolved: the interval excludes zero, and the point estimate is 28.4% lower than top-p. The power-decoder arm gives a complementary smooth-decoder result, but the three rows define different decoding targets, so they are not an equal-strength or answer-quality ranking. Section 5.4 (pp. 9–10) and Appendix I (p. 26) report all three arms.

Question 2, whether smoothness guarantees invariance. We acknowledge the distinction between reducing drift and eliminating representation dependence. The tested mixture retains a hard truncation component unless its full-sampling weight reaches 100%.

Even a fully smooth decoder can depend on representation. Consider power decoding with exponent 2, which squares each probability and then renormalizes. Starting with two equally likely outcomes (0.5, 0.5), the decoded distribution remains unchanged. However, if the first outcome is split into two labels, each with probability 0.25, while the second remains a single label with probability 0.5, applying power decoding to the labels and then merging them produces (1/3, 2/3), rather than (1/2, 1/2).

Thus, smoothness alone does not guarantee representation invariance. Our measured attenuation and the exact identity in Equation (23) demonstrate that drift can be reduced without an explicit quotient, while quotient-first decoding guarantees preservation of the specified outcome law.

Appreciate your comments and questions.

Thank you for your detailed and transparent rebuttal.

Your new experimental and theoretical explanations directly answered all my technical questions—in particular, the ARC-Challenge and GSM8K benchmarks clarified the impact on downstream tasks.

However, considering all the newly reported results—including natural same-support distortion (< 4.6 × 10⁻⁹) and statistically indistinguishable benefit on downstream tasks—the impact on practical LLM tasks seems rather limited.

While I still appreciate the rigor of the theoretical analysis, I have adjusted my rating from 4 to 2 (Weak rejection) to better reflect its practical applicability.

Thank you for the thoughtful follow-up, your recognition of the theoretical rigor, and your confirmation that our responses answered your technical questions. Your feedback has helped us make the practical contribution more concrete: the revised paper connects its guarantees to implementation checks, measurable changes in generated responses, and a tested way to reduce representation sensitivity.

The practical contribution is a way to verify and control a specified sampling policy. Quotient-first decoding has a clear operational goal: recover the application's chosen parent-level sampling law when several labels represent the same outcome. In the full ARC-Challenge and GSM8K evaluation on Qwen2.5-0.5B-Instruct, parent-first and quotient-first match on all 2,491 coupled saved paths. The exact guarantee follows from the construction, and these checks confirm its faithful implementation in this evaluation.

The natural terminal-answer study provides a useful calibration point. For legal one-token answer aliases, conditioned on legal answers and with generation stopping after the selected label, the mean same-support distortion is below 4.6×10−94.6\times10^{-9}. Section 5.4 identifies this low-sensitivity setting. The analytical contribution makes such assessments systematic: Proposition 2.1 tests whether the actual encoding preserves the intended law, and Theorem 3.1 gives the exact largest same-support distortion from the original nucleus. A designer can therefore check an implementation and set a quantitative error budget without enumerating possible encodings.

The additional evaluations reveal measurable consequences in generated text. Your original diversity question is addressed by the separate full-GSM8K study in Appendix J.3 and Tables 16–17: all 1,319 questions, four outputs per question and policy, and a common 1,024-token budget, giving 63,312 outputs across three models and four policies. The measure is pairwise cosine distance between chunk-averaged frozen MPNet embeddings of full responses, including invalid and capped outputs. Seven of nine comparisons remain resolved after Holm adjustment using 20,000 paired question-bootstrap resamples, with the direction depending on the model and policy. For example, Qwen3 uniform refinement lowers this dispersion proxy by 0.00376, with paired 95% interval [−0.00461, −0.00293]. This connects the distributional analysis to an observable property of generated responses and gives designers evidence about response variability alongside answer correctness.

There is also a concrete, tested way to reduce representation sensitivity. The additional attenuation panel directly addresses your suggestion of modifying hard truncation without requiring an explicit quotient. At each step, the mixture uses full sampling with probability 0.25 and top-p with probability 0.75. Its implementation requires no grouping of equivalent outcomes.

The controlled comparison uses 30 matched prompt families, ten each from ARC-Challenge, GSM8K, and MMLU, two generation seeds, both sampling lanes, uniform and Dirichlet eight-way refinement, temperature 0.7, and top-p 0.9. Mean parent-path TV at a 128-token horizon is:

ModelRefinementTop-p TVMixture TVPaired change [95% CI]
Qwen3-8BDirichlet0.3800.251−0.129 [−0.204, −0.055]
Qwen3-8BUniform0.4090.271−0.138 [−0.192, −0.083]
Qwen2.5-0.5B-InstructDirichlet0.4560.278−0.178 [−0.247, −0.107]
Qwen2.5-0.5B-InstructUniform0.4200.289−0.132 [−0.182, −0.079]
Olmo 3 7B InstructDirichlet0.3610.243−0.118 [−0.178, −0.059]
Olmo 3 7B InstructUniform0.4600.347−0.113 [−0.159, −0.066]

All six reductions survive Holm adjustment over 24 endpoint contrasts. The nominal paired 95% intervals use 20,000 task-stratified family-bootstrap resamples, averaging seeds and lanes within family and weighting tasks equally. Each TV column measures the sensitivity of its stated sampling policy. Equation (23) gives the exact one-step attenuation; Appendix J.2 and Table 15 report the measured path effects. These consistent reductions provide an implementable option for controlling sensitivity across all six tested model/refinement settings.

Together, these results provide a clear route from analysis to decoder design: test whether the intended probabilities are preserved, quantify the possible distortion, and choose an appropriate way to control it. We hope this makes the practical value of the contribution clearer. Thank you again for the thoughtful discussion. We would be grateful if you could reconsider your revised score in light of the exact guarantees and the evidence addressing your diversity and attenuation questions. Appreciate it.

Reviewer_6GsfOpenReview ↗
Rating
2
Confidence
2
Informativeness
1
Presentation
1
Soundness
2
Read review
Paper summary

The paper explores truncation decoder in language models and how refinement processes to decoder can affect the final probability distribution. Particularly, the paper explores how top-p sampling can change output probabilities when the probability mass is split into smaller virtual children. They state that the output probability can change even when all possible outcomes can remain possible. While the authors state quotient-first decoding as a simple remedy, their main contribution is not the method, rather theoretical characterization of the problem and the remedy. Particularly the authors provide a detailed characterization analysis for truncation decoder and the conditions for preserving the outcome distribution.

Critical strengths
  • The paper’s main strengths are the theoretical characterizations of truncation decoder. The analyses appear mathematically sound, and the characterization results, sharp bounds, and accompanying constructions provide good observation of how refinement affects such decodings.
  • The paper’s controlled experiments support their analysis well across multiple language models.
Critical weaknesses
  • The paper’s algorithmic novelty appears limited. While the characterizations are strong, the remedy ‘quotient-first decoding’ is not a new method as the authors acknowledged (line 083). This creates a gap in the main contribution and appears to me as limited. The manuscript could explore more how their results can provide useful directions for designing better and practical decoding systems.
  • While the paper’s characterization analysis is strong, the reason for such analysis and real-world usage impact is unclear to me. The paper doesn’t mention or connect a useful research problem to motivate why such analysis is needed.
  • The paper’s misses out cruicial details of the reseach problem and motivation in earlier sections. The abstract and introduction sections could make a more concrete motivation behind their exploration.

Due to these reasons I’m leaning toward a weak rejection.

Questions for authors

None

6 comments
AuthorsOpenReview ↗

Algorithmic novelty and useful decoder-design directions

The established remedy versus the new characterization. Thank you for distinguishing the sound characterization from the algorithmic contribution. We agree that aggregate–decode–condition sampling is established. Our novelty is the complete reachable-law characterization, its common convex-divergence extremizer, and sharp support-constrained local and path limits. A known coherent implementation does not itself determine every distortion attainable by the opposite order.

The decoder-design directions requested in Weakness 1. Thank you for asking us to make the consequences operational. These results translate directly into four decoder-design decisions. First, the application defines which labels count as one outcome; this is the grouping supplied to the theory. Second, Proposition 2.1 tests invariance through retained fractions, and Theorem 3.1 computes the largest possible same-support distortion from the original nucleus alone. Third, when preserving that outcome law is required, aggregating before truncation removes the distortion exactly. Fourth, for approximate aggregation, Corollary B.5 supplies a local error certificate under its rank and threshold margins. When no grouping is available, a full-sampling mixture instead attenuates drift without guaranteeing invariance.

The quantitative decision rule. We appreciate the request for a usable criterion, rather than only an abstract characterization. With equal retained supports, the laws agree if and only if their retained fractions are equal across outcomes. A support-only check can therefore pass while probabilities change. The exact largest same-support TV error is

Sk−1(Sk−ρ)ρSk,\frac{S_{k-1}(S_k-\rho)}{\rho S_k},

where Sj=∑i≤jpiS_j=\sum_{i\le j}p_i and the parent nucleus contains the first kk outcomes. If this bound is below the application's tolerance, every admissible same-support refinement meets it. Otherwise, the constructive theorem identifies an attainable distortion at the bound. The same extremal law maximizes every convex f-divergence.

The clarification and supporting evaluation. Thank you for connecting novelty to practical usefulness. We have added the explicit diagnostic, error budget, and approximation certificate to Section 4 (p. 6), with the full certificate in Corollary B.5 (p. 22). The additional matched 60-family Qwen3-8B panel also provides a statistically supported mitigation option:

DecoderMean parent-path TVPaired change
Top-p(0.9)0.218Reference
25% full-sampling mixture0.156−0.0618 [−0.0897, −0.0351]

The paired interval excludes zero, so the result directly supports attenuation under this protocol. Section 5.4 and Appendix I report the protocol and distinguish attenuation from exact preservation. This directly addresses what the characterization changes for decoder analysis and design, beyond the established sampling construction.

AuthorsOpenReview ↗

Research motivation, practical meaning, and the opening explanation

Weakness 2: why is this a useful research problem? Thank you for asking us to state the problem up front. Consider several legal terminal labels mapped to the same selected action. Their combined model probability is the probability assigned to that action. Truncating labels separately can change it merely because the mass is divided differently, even when every retained outcome remains possible. The research question is whether a decoder preserves the application's chosen outcome law and, if not, how large the representation-induced error can be. Our characterization answers both questions without requiring every application to merge its labels.

Weakness 2, evidence for the mechanism. We appreciate your request to connect the analysis to real model behavior. The controlled experiment holds weights, tokenizer, and the untruncated kernel fixed at a shared history by feeding back only parent tokens. Uniform eight-way refinement reaches mean parent-path TV 0.256 [0.245, 0.267] across 120 Qwen3-8B families at 64 tokens. Thus random split imbalance and support deletion are unnecessary. This retained experiment measures sensitivity to decoder order, not an accuracy gain.

Weakness 2, additional evidence for task consequences. Thank you for raising practical impact; to measure it directly, we added the full-task evaluation also requested by 9EtP. Qwen2.5-0.5B-Instruct is evaluated on all 1,172 ARC and 1,319 GSM8K questions.

PolicyARC-Challenge accuracyGSM8K accuracy
Parent-first top-p40.27%37.00%
Quotient-first40.27%37.00%
Uniform refinement40.78%38.21%
Dirichlet refinement40.36%37.68%
Greedy43.43%43.29%

Both refinement policies have slightly higher point estimates than parent-first on both tasks. For uniform refinement, the paired differences are +0.51 percentage points on ARC [−0.26, 1.37] and +1.21 on GSM8K [−0.83, 3.26]. Neither refinement differs significantly from parent-first after Holm adjustment over 20 paired comparisons; the intervals condition on the checkpoint and single stochastic seed. All 2,491 coupled parent/quotient-first saved paths match as an implementation check, not a proof of universal identity. The result therefore does not establish an accuracy gain, but it also does not reveal a statistically distinguishable accuracy penalty under this protocol. Section 5.3 and Table 2 (p. 9), with Appendix H (p. 26), report the complete comparison. This separates preservation of a chosen law from accuracy optimization.

Weakness 3: the abstract and introduction need concrete motivation. Thank you for identifying that the basic operation needed to appear earlier. We have rewritten the abstract and added the opening example (p. 1): splitting each mass in (0.6,0.3,0.1)(0.6,0.3,0.1) into three equal labels changes the top-p(0.8) outcome law from (2/3,1/3,0)(2/3,1/3,0) to (3/4,1/4,0)(3/4,1/4,0) without losing an outcome. Section 4 (p. 6) then explains the invariance test and error budget. These changes directly address your motivation, accessibility, and practical-value concerns.

We would appreciate reconsideration on that clarified basis. Thank you.

Reviewer_6GsfOpenReview ↗

Response to authors

Thank you for taking your time to respond to my review. After careful reading the response, I am not convinced how the problem being explored adds value to real world scenario to be worthy of a contribution. Furthermore, most of my concerns are remained unaddressed, whereas I feel that the response addresses questions that I never asked. Because of these reasons, I want to retain my score. I appreciate the authors' effort.

Comments on the paper

2 comments
AuthorsOpenReview ↗

Clarified contribution, three additional evaluations, and a clearer opening

We thank 6Gsf, 6H3V, vvMo, and 9EtP for their constructive feedback. We have added three evaluations: task accuracy, attenuation without an explicit quotient, and native terminal-action sensitivity. These answer 9EtP's accuracy and attenuation questions and clarify the practical scale raised by 6Gsf, 6H3V, and vvMo. The central contribution remains an exact characterization, rather than a new aggregate-first sampling wrapper.

Novelty and design value, addressing 6Gsf and vvMo. Thank you for asking what the theory changes for decoder design. Theorem 3.1 identifies every attainable same-support law at a fixed distribution and one maximizer for every convex f-divergence; Theorem 3.2 gives sharp local and path limits. We have made the consequence explicit: test retained fractions for invariance, compute the exact worst-case error, and aggregate first when the application requires preservation. Section 4 (p. 6) states this diagnostic and error budget.

Task accuracy, addressing 9EtP and the practical-impact concerns of 6Gsf and 6H3V. Thank you for requesting direct task evidence. We evaluated Qwen2.5-0.5B-Instruct on all 1,172 ARC-Challenge and 1,319 GSM8K questions under five policies.

PolicyARC-Challenge accuracyGSM8K accuracy
Parent-first top-p40.27%37.00%
Quotient-first40.27%37.00%
Uniform refinement40.78%38.21%
Dirichlet refinement40.36%37.68%
Greedy43.43%43.29%

Interpretation. Quotient-first matches parent-first on all 2,491 coupled saved paths, an implementation check; exact coherence follows from the construction. Uniform-minus-parent is +0.51 percentage points on ARC [−0.26, 1.37] and +1.21 on GSM8K [−0.83, 3.26], but neither refinement differs after Holm adjustment. The evaluation therefore finds no statistically distinguishable accuracy change under this single-seed protocol. Section 5.3 and Table 2 (p. 9) report the comparison.

Attenuation, addressing 9EtP's Question 2. Thank you for asking whether drift can be reduced without specifying a quotient. The matched 60-family panel gives a clear positive attenuation result:

DecoderMean parent-path TVComparison with top-p
Top-p(0.9)0.218Reference
25% full-sampling mixture0.156−0.0618 [−0.0897, −0.0351]
Power decoder, exponent 1.250.0381 [0.0335, 0.0429]Separate smooth decoding target

The mixture's paired interval excludes zero, directly supporting attenuation. The power decoder is a separate target, not an equal-strength or answer-quality comparison. Section 5.4 and Appendix I distinguish both results from exact invariance.

Natural scale and accessibility, addressing vvMo and 6H3V. Thank you for requesting a concrete setting and a gentler explanation. The terminal-action study covers full ARC/MMLU populations on three models and identifies a low-sensitivity natural setting: mean one-step TVs range from 5.7×10−55.7\times10^{-5} to 1.3×10−31.3\times10^{-3} and are driven by rare support changes. Section 5.4 contrasts this scoped finding with the controlled uniform-refinement result, TV 0.256 [0.245, 0.267] without support loss across 120 Qwen3 families. The revised abstract and opening example (p. 1) explain splitting before notation. These additions preserve the contribution and directly address the practical and presentation concerns.

Thank you for the continued discussion. We would like to highlight three additional evaluations beyond the results in our first two replies. Here we explain what they add to vvMo's and 6Gsf's questions about decoder design and to 6H3V's question about the size and practical meaning of the effect. The repeated-decoding study measures how the effect changes when the decoder is used throughout generation. Appendix J reports all three studies.

1. New repeated-decoding comparison. We varied how often the representation-sensitive operation is applied: at the first step only, every fourth step, after step 32, or at every step. Each model uses 60 fixed prompt families, 20 each from ARC-Challenge, GSM8K, and MMLU, four generation seeds, both sampling lanes, uniform eight-way refinement, temperature 0.7, and top-p 0.9. Mean parent-path TV at 64 tokens is shown below:

ModelFirst step onlyEvery fourth stepAfter step 32Every step
Qwen3-8B0.00950.1020.1520.249
Qwen2.5-0.5B-Instruct0.03780.1290.1540.265
Olmo 3 7B Instruct0.01550.1280.1700.289

In all twelve settings, the measured discrepancy comes from reweighting shared paths; the recorded one-sided-support contribution is zero. For Qwen3, the first-step-only and every-step 95% intervals are [0.0049, 0.0148] and [0.230, 0.269]. This shows that a first-step diagnostic can substantially understate sensitivity when the operation is applied repeatedly. Appendix J.1 and Table 14 report these descriptive comparisons of complete schedules. These results give decoder designers a concrete reason to assess sensitivity over the full sequence, alongside the local diagnostic.

2. A practical way to reduce representation sensitivity. In a separate matched panel, we use 30 fixed families, two generation seeds, both sampling lanes, eight-way refinement, temperature 0.7, top-p 0.9, and a 128-token horizon. We compare top-p with its 25% full-sampling mixture:

ModelRefinementTop-p TVMixture TVPaired change [95% CI]
Qwen3-8BDirichlet0.3800.251−0.129 [−0.204, −0.055]
Qwen3-8BUniform0.4090.271−0.138 [−0.192, −0.083]
Qwen2.5-0.5B-InstructDirichlet0.4560.278−0.178 [−0.247, −0.107]
Qwen2.5-0.5B-InstructUniform0.4200.289−0.132 [−0.182, −0.079]
Olmo 3 7B InstructDirichlet0.3610.243−0.118 [−0.178, −0.059]
Olmo 3 7B InstructUniform0.4600.347−0.113 [−0.159, −0.066]

All six reductions survive Holm adjustment over 24 endpoint contrasts, covering four nonzero mixture weights per model/refinement cell. The nominal paired 95% intervals use 20,000 task-stratified family-bootstrap resamples. Both path studies average seeds and lanes within each family and then weight tasks equally. Appendix J.2 and Table 15 report the comparison. These consistent reductions extend the earlier single-model result and give designers a tested way to reduce representation sensitivity across all six model/refinement settings.

3. What changes in the generated responses. We evaluated all 1,319 GSM8K questions with four outputs per question and policy and a common 1,024-token budget, for 63,312 outputs across three models and four policies. Mean pairwise cosine distances between chunk-averaged frozen MPNet embeddings of the full responses are:

ModelParent top-pUniformDirichletFull sampling
Qwen3-8B0.03690.03310.03480.0401
Qwen2.5-0.5B-Instruct0.2290.2320.2200.225
Olmo 3 7B Instruct0.04170.03900.04060.0475

Both refinements lower this dispersion proxy for Qwen3 and Olmo, while full sampling increases it. For Qwen2.5, the Dirichlet contrast decreases the proxy, while the uniform and full-sampling contrasts remain unresolved after adjustment. For example, Qwen3 uniform minus parent is −0.00376 [−0.00461, −0.00293]. The analysis uses 20,000 paired question-bootstrap resamples and Holm adjustment over nine contrasts. Questions are the resampling units. The metric measures dispersion across all responses, including invalid and capped outputs. Appendix J.3 and Tables 16–17 report all comparisons. This connects the distributional analysis to a measurable property of generated text and clarifies what changes when the decoder changes.

These additions make the design implications and measured scale clearer, complementing the earlier task-accuracy and natural terminal-action studies. Thank you again for reviewing our work. We hope these additional results and clarifications address your questions, and we would appreciate it if you could revisit our responses and reconsider your evaluation.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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