acceptodds
Withdrawn from ICLR 2027

Minimal Sufficient Skills: Information-Bottleneck Evolution of Procedural Knowledge

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Large language model agents use reusable skills to encode procedural knowledge for specialized, multi-step tasks. Existing skill-evolution methods refine these artifacts using execution feedback but focus primarily on adding or revising content, without identifying which components are necessary for transferable behavior. Evolved skills can therefore accumulate obsolete rules, redundant procedures, instance-specific details, and verifier-dependent content. Conventional length penalties and free-form summarization cannot distinguish dispensable tokens from behavior-critical instructions. We introduce MSS, a framework for identifying minimal sufficient procedural knowledge under explicit behavioral constraints. MSS formulates skill evolution as a multi-objective search that jointly considers task reward, description length, dependence on construction instances, and preservation of transferable behavior. Its deletion-first procedure removes candidate modules, merges equivalent rules, abstracts examples into task-level invariants, and eliminates verifier-specific content before adding new information. Module-level counterfactual tests accept a reduction only when the targeted behavior remains supported under the prescribed validation conditions. This process jointly compresses textual instructions and executable utilities. The resulting Pareto frontier characterizes the trade-off between compactness and behavioral sufficiency without imposing a single unconstrained skill-selection criterion. We analyze this frontier using skill information density, behavior-per-token, and compression robustness, and define an evaluation protocol covering in-distribution performance, cross-task transfer, cross-model reuse, and robustness to tool perturbations. This formulation treats skill compression as behavior-preserving procedural reduction beyond surface-level shortening.

Primary area:
applications to computer vision, audio, language, and other modalities
Keywords:
Minimal Sufficient Skills, Procedural Knowledge Compression, Behavior Preservation

Reviews

Among:
Shape:
1234this paper, Bottom 2%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.33 over 3 reviews, above 2% of the others.
Reviewer_ZhTGOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
1
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Paper summary

This paper introduces Minimal Sufficient Skills (MSS), a deletion-first framework for evolving compact agent skills while preserving task behavior. MSS decomposes skills into dependent modules, proposes structured deletions and abstractions, and accepts edits using counterfactual validation, instance-dependence estimates, and Pareto selection. Experiments on four author-curated task groups report improved held-out performance, transfer robustness, and skill compression relative to several author-defined control baselines. However, the task suite and experimental details are not sufficiently specified for independent reproduction, and the paper does not directly compare MSS with existing skill-evolution systems discussed in the literature.

Critical strengths
  1. The paper presents a clear motivation for behavior-preserving skill compression. The deletion-first design and counterfactual checks are reasonably aligned with this objective.
  2. The experiments include several component ablations and transfer settings. These analyses provide some evidence that the proposed design choices affect the reported results.
Critical weaknesses
  1. Evaluation is restricted to an underspecified, author-curated dataset. The paper evaluates only on four internally constructed task groups and does not provide a sufficiently precise public specification of the instances, task-generation procedure, initial skills, verifiers, or data release. The main experimental section also does not clearly identify the backbone models and other experimental settings in a centralized, reproducible way. No results are reported on established public benchmarks such as SkillsBench, SpreadsheetBench, OfficeQA, or ALFWorld. This makes it difficult to reproduce the study and raises concerns that the chosen tasks, verifiers, and skill distributions may favor MSS or make the reported comparisons unfair.
  2. There is no direct comparison with the skill-evolution methods discussed in Related Work. The paper explicitly discusses SkillEvolver [1] and SkillRL [2], but neither method is included in Table 1. The reported baselines are mostly author-defined controls (random deletion, token penalty, LLM summarization, and a generic incremental-editing prompt), rather than reproductions of published systems. The paper should also consider representative recent works such as SkillOpt [3], Trace2Skill [4], and EvoSkill [5], using a common public benchmark and matched budgets. Without these comparisons, the claim that MSS improves over existing skill-evolution approaches is not supported.

Refs:

[1] SkillEvolver: Skill Learning as a Meta-Skill.

[2] SkillRL: Evolving Agents via Recursive Skill-Augmented Reinforcement Learning.

[3] SkillOpt: Executive Strategy for Self-Evolving Agent Skills.

[4] Distill Trajectory-Local Lessons into Transferable Agent Skills.

[5] EvoSkill: Automated Skill Discovery for Multi-Agent Systems.

Questions for authors

Please see weaknesses.

Reviewer_PrTTOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

The paper argues that skill-evolution methods mostly add content, which produces bloated skills containing obsolete rules, duplicates and instance- or verifier-specific details. It proposes Minimal Sufficient Skills (MSS). MSS applies deletion-first operators (deletion, merging, abstraction and sanitization) to dependency-closed modules. An edit is accepted only after counterfactual audits of reward, behaviour and robustness, and the final skill is selected from a Pareto archive. The evaluation uses a curated four-group benchmark with a Qwen2.5-72B-Instruct backbone. There, MSS reportedly compresses a 3.84K-token skill to 1.46K tokens while raising the OOD pass rate from 50.8 to 57.6.

Critical strengths

S1. The paper tackles a relevant problem with an appealing idea. Skill bloat and overfitting to construction instances are real concerns for self-evolving agents. Recasting delta debugging as a deletion-first search is a neat idea. It complements the predominantly additive evolution methods.

S2. The acceptance criteria are more principled than plain shortening. Each edit is audited jointly for reward, behaviour signatures and robustness under perturbation. Deletion is dependency-closed across both text and code modules. Together, these are better motivated than length penalties or free-form LLM summarization.

Critical weaknesses

W1. The evaluation benchmark is insufficiently described, which makes the results hard to interpret. App. B.1 describes "a curated agent-skill benchmark" but does not give its source, construction procedure or verifiers. The paper also does not explain how the 3.84K-token initial skills were obtained. Every conclusion rests on this benchmark, so I would ask the authors to describe it in detail and to add evaluation on public benchmarks such as SkillsBench.

W2. The description of the experimental protocol contains multiple inconsistencies. The seeds are {0–4} in App. B.2 but 13/21/42/87/100 in Table 10. Table 8 uses up to 60 audit instances, although each group has only 10 validation and 30 evolution instances. The selection rule is the BPT knee point in Sec. 3.4 but the shortest near-best candidate in Sec. 4.1, and BPT is computed from the audit reward in Eq. 7 but from the OOD test pass rate in B.2. The evaluator is said to use "no learned judge" (B.3), yet D.8.3 gives an LLM prompt returning task_passed. Sec. 4.4 also claims performance stays "within one point" at about 50% compression, contrary to Table 5 (56.9 vs. 50.8). Please reconcile these points and provide per-seed, per-instance logs.

W3. The source of the large performance gains is not explained. Edits are accepted only if they do not degrade the audit reward. Yet MSS improves the OOD pass rate by 6.8 pp and ID performance by 3–6 pp in every domain, and the paper should show which deletions drive these gains. It is also unclear why the additive baseline ends shorter (3.06K tokens) than the initial skill (3.84K), and why all three metrics in Table 10 increase monotonically with the seed index. The paired bootstrap in Table 11 should also state how many OOD instances it is based on.

W4. The information-bottleneck framing is largely nominal, and the comparisons are dated. No IB objective is actually optimized. Eq. 6 is a classifier likelihood ratio over surface identifiers, and selection amounts to constrained length minimization. In addition, the only backbone is Qwen2.5-72B-Instruct, and the paper compares against no recent skill-optimization method, such as ACE, GEPA or SkillOpt.

W5. The presentation, especially the figures, needs improvement. The abstract reports no results, and Figures 1 and 2 share an identical caption. Both figures are embedded as low-resolution raster images in a style (generic icons and decorative symbols) suggesting they may have been produced with an AI image-generation tool. The AI disclosure, however, mentions only language editing. If this is the case, I would kindly ask the authors to update the disclosure and to check every element of the figures against the method. Redrawing the figures as vector graphics would also improve legibility. Finally, citation formatting is broken in places, and the disclosure refers to "theoretical proofs" that the paper does not contain.

Questions for authors

Please see the Weaknesses section.

Reviewer_WHsrOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

This paper proposes Minimal Sufficient Skills (MSS), a framework for compressing agent skills while preserving task performance, behavioral signatures, and robustness. Skills are decomposed into dependent text and code modules, modified through deletion, merging, abstraction, and sanitization, and evaluated using paired executions. Accepted candidates enter a Pareto archive. Experiments report improved performance and reduced skill length across four task families. The problem is relevant, but I have substantial concerns about the mathematical formulation and inconsistencies in the experimental protocol. These prevent a reliable assessment of the central claims.

Critical strengths
  1. The paper addresses a practical problem. Evolving skills can accumulate redundant rules, contradictory instructions, instance-specific details, and obsolete utilities. Removing these while preserving execution-critical behavior is a worthwhile objective.

  2. Several design choices are sensible. Dependency-aware edits reduce invalid artifacts, paired executions improve comparability, and the reference-relative constraints in Appendix A address the accumulation of small parent-relative degradations. The qualitative examples illustrate why compression should preserve operational constraints rather than merely shorten prose.

Critical weaknesses

1. Equation (6) does not establish the intended instance-dependence penalty.

For a fixed skill ss, Equation (6) averages the log probability ratio over evolution-instance identities while supplying the same h(s)h(s) to the classifier for every term. Under the stated uniform prior and a normalized classifier distribution, this is the negative KL divergence:

Dinst(s)=−DKL(p∥qψ(⋅∣h(s)))D_{\mathrm{inst}}(s) = -D_{\mathrm{KL}}(p \parallel q_\psi(\cdot \mid h(s))).

It is therefore nonpositive, and minimizing it rewards departures from the uniform prior rather than the intended suppression of instance-identifying information.

For example, with two instances, a uniform prediction gives zero, whereas a prediction of (0.9, 0.1) gives approximately -0.511 using natural logarithms. The latter is preferred by the stated minimization objective.

This also does not constitute the claimed mutual-information estimate without an appropriately specified joint sampling relationship between skills and construction instances. If the implementation uses a different statistic, both the definition and its connection to the reported results require correction.

2. The reported audit configuration is inconsistent with the main results.

Section 4.1 and Appendix B describe ten validation instances per task group, and Appendix B.3 states that candidates are screened on all ten. However, Table 8 reports 55.9% OOD performance and 1.39K tokens for ten audit instances. The main result of 57.6% and 1.46K tokens instead matches the thirty-instance setting.

The paper does not explain whether the main experiment used ten or thirty audit instances, or where additional audit instances originated. This affects the interpretation of data separation, validation budgets, and comparisons between methods. The inconsistency must be resolved with an explicit account of the actual runs.

3. Candidate selection and metric definitions are not consistent across sections.

Section 3.4 selects a candidate by maximizing a behavior-adjusted BPT score, described as a knee point. Section 4.1 and Appendix B.3 instead select the shortest feasible candidate within one percentage point of the best validation pass rate. These rules can select different artifacts.

Likewise, Equation (7) includes a behavioral-deviation factor, whereas the experimental BPT is defined as OOD pass rate divided by skill length in thousands of tokens. The paper should distinguish an audit-time selection criterion from a test-time reporting metric and identify which criterion was actually used. At present, the formal objective and experimental procedure are insufficiently aligned.

4. The evaluation statistics require clarification.

Appendix B.2 specifies seeds {0,1,2,3,4}\{0, 1, 2, 3, 4\}, whereas Table 10 lists {13,21,42,87,100}\{13, 21, 42, 87, 100\}, without explaining separate roles for these sets.

The reported pass rates also do not readily follow from the stated sample sizes. If each domain contains thirty binary test instances evaluated once under each of five seeds, the mean domain pass rate changes in increments of approximately 0.667 percentage points. Values such as the reported 60.5% spreadsheet ID result cannot arise under that aggregation scheme after rounding to one decimal place. Additional repetitions or another aggregation procedure could explain this, but neither is specified. Per-instance outcomes and exact evaluation denominators are needed to verify the results.

5. The minimality and information-bottleneck claims exceed what is established.

The search terminates after a limited number of rounds, archive stagnation, or budget exhaustion. This returns a compact feasible candidate, but does not establish global minimality or clearly guarantee one-minimality with respect to the remaining modules. The paper appropriately qualifies sufficiency as empirical, but should apply comparable precision to minimality.

More broadly, the mechanism is closely related to test-driven reduction and constrained search. A convincing contribution would require a valid instance-dependence formulation, an unambiguous implementation, and reliable evidence that the additional machinery improves over dependency-aware reduction under matched resources. The current reporting does not support that conclusion confidently.

Questions for authors
  1. Is Equation (6) implemented literally? If so, how is its minimization reconciled with its negative-KL form? If not, what statistic is actually used?
  2. Did the main experiments use ten or thirty audit instances per task group? Where did the additional audit instances come from?
  3. Which final selection rule produced the reported skills: maximum behavior-adjusted BPT or shortest-within-one-point selection?
  4. What are the exact evaluation denominators, rollout counts, seed roles, and aggregation procedures underlying the pass rates?
  5. Can the authors provide the task suite, initial skills, frozen probe, and per-instance execution results?6. What minimality property, if any, is guaranteed when the search terminates?

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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