acceptodds
Under review as a conference paper at ICLR 2027

When Successful Strategies Fail: Adaptation to Environmental Novelty in Terminal Agents

Abstract

LLM agents increasingly solve long-horizon tasks by autonomously interacting with their environment. In doing so, their strategies rely on assumptions about that environment: which resources and tools exist, where they are located, and how they behave. When these assumptions no longer hold, reliable agents must detect the change and adapt while pursuing the same goal. We study this *adaptation capability* through *environmental novelty*: a change that keeps the task objective fixed while invalidating an assumption underlying an otherwise successful trajectory. We introduce AGNI, an automated pipeline that extracts trajectory-relevant assumptions, injects targeted environmental changes, and validates that the resulting novel tasks remain solvable. Across three terminal benchmarks, AGNI produces diverse novelties spanning resources, interfaces, constraints, and execution semantics. Evaluating multiple LLM agents reveals a substantial adaptation gap between base and novel tasks. Trajectory analysis suggests that agents often encounter evidence of the change but fail to localize its cause, revise their strategy, or verify recovery. Finally, post-training on environmental novelty improves adaptation on held-out novel tasks while also improving performance on base tasks. Our results highlight a gap between task competence and adaptive capability and motivate environmental variation as a core dimension of agent training and evaluation.

Primary area:
foundation or frontier models, including LLMs
Keywords:
environmental novelty, agent evaluation, LLM agents, terminal agents, adaptation, robustness, post-training

Reviews

Among:
Shape:
1234this paper, Top 4%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.33 over 3 reviews, above 96% of the others.
Reviewer_4asxOpenReview ↗
Rating
3(+1)
Confidence
3
Informativeness
2(+1)
Presentation
2
Soundness
2(+1)
Read review
Paper summary

This paper studies whether LLM-based terminal agents can adapt when environmental changes break their previously successful strategies. The authors introduce AGNI, a pipeline that automatically generates controlled base–novel task pairs by identifying implicit assumptions in successful trajectories and invalidating one such assumption while preserving task solvability.

Critical strengths
  1. The problem of environmental novelty in terminal agents is well motivated, grounded in realistic software-evolution scenarios where implicit assumptions routinely break.

  2. The formalization and the AGNI pipeline are described clearly.

Critical weaknesses
  1. AGNI and the post-training interventions combine existing LLM capabilities and known techniques into a pipeline, making the trajectory-derived versus predefined-perturbation distinction an engineering improvement rather than a new algorithmic or theoretical contribution.

  2. AGNI partitions environmental novelty into certain categories without justifying why these four dimensions are sufficient or characterizing what classes of real-world environment changes fall outside this taxonomy.

  3. The formalization invalidates exactly one assumption per task pair, but real software changes often break multiple interdependent assumptions at once, and the paper does not establish whether the bidirectional oracle validation remains sound when correlated assumptions fail together or whether it may accept pairs whose success depends on an unintended secondary violation.

  4. The pipeline is conditioned on the analyzer model's extraction of trajectory-relative assumptions, yet no precision estimate or error taxonomy is reported for this step, so if the analyzer systematically over-generalizes or misattributes assumptions the oracle check cannot detect the misalignment.

Questions for authors
  1. AGNI partitions environmental novelty into four categories without justifying why these dimensions are sufficient. Could the authors clarify whether this taxonomy is derived from a prior framework or induced empirically, and characterize what classes of real-world environment changes fall outside it?

  2. The formalization invalidates exactly one assumption per task pair, but real software changes often break multiple interdependent assumptions at once. Could the authors clarify whether the oracle validation remains sound when correlated assumptions fail together?

  3. The entire pipeline is conditioned on the analyzer model's extraction of trajectory-relative assumptions, yet no precision estimate or error taxonomy is reported for this step.

  4. The reported gains in novel pass@1 are difficult to attribute to a genuine capability for diagnosing environmental changes and revising strategy, since both the training and evaluation novelties are constructed by the same GPT-5.5 analyzer over similar task distributions. The trained model may instead be acquiring shortcuts that memorize AGNI-style novelty patterns or produce meta-action labels as a formatting artifact, rather than learning general adaptation.

4 comments
AuthorsOpenReview ↗

C1–C3: Methodological Contributions, Novelty Dimensions, and Validation Scope

Thank you for your thoughtful review and for raising several interesting points. We appreciate your recognition that the problem of environmental novelty in terminal agents is well motivated and that our formalization and AGNI pipeline are clearly described. We address your specific concerns below:

C1. AGNI and the post-training interventions combine existing LLM capabilities and known techniques into a pipeline, making the trajectory-derived versus predefined-perturbation distinction an engineering improvement rather than a new algorithmic or theoretical contribution.

We agree that our work builds on existing techniques, but this does not diminish our methodological and empirical contributions, which are also recognized by the other reviewers.

Our primary contribution is a methodology to systematically study and improve adaptation in terminal agents. To this end, we introduce AGNI, which enables scalable construction of environmental novelties in heterogeneous, open-ended terminal tasks. Unlike predefined perturbations, AGNI derives novelties from assumptions underlying successful agent strategies, making them specific to the task and strategy (Section 4). We use this setup to evaluate adaptation across models, analyze failure modes, and investigate how post-training can improve adaptation (Sections 5–6).

Adaptation is critical to the reliability of autonomous coding agents. An agent that stops upon encountering an unexpected condition provides a worse user experience than one that identifies its cause, revises its strategy, and completes the task (Figure 1). Our methodology enables us to systematically study and improve this important capability.

C2. AGNI partitions environmental novelty into certain categories without justifying why these four dimensions are sufficient or characterizing what classes of real-world environment changes fall outside this taxonomy.

Our four novelty dimensions are conceptually motivated by the POMDP formulation (Williams & Young, 2007). POMDPs model agent-environment interaction in terms of observations, actions, and state transitions. Motivated by this formulation, we organize novelties according to how they interfere with these components: changing what agents observe (perception), how they act (control), which actions are feasible (constraints), and how the environment responds to their actions (dynamics). These four dimensions are defined a priori and serve as broad, non-exhaustive categories for organizing and generating novelties (Algorithm 1, lines 4–7).

We will clarify this motivation and scope in the revised paper.

Williams & Young. Partially Observable Markov Decision Processes for Spoken Dialog Systems. Computer Speech & Language, 2007.

C3. The formalization invalidates exactly one assumption per task pair, but real software changes often break multiple interdependent assumptions at once, and the paper does not establish whether the bidirectional oracle validation remains sound when correlated assumptions fail together or whether it may accept pairs whose success depends on an unintended secondary violation.

We deliberately target one trajectory-relative assumption per novel task pair to support a controlled study of adaptation, but this does not require that no other assumptions be affected.

AGNI's validation checks that the original oracle solution fails, an adapted oracle solution succeeds, and successful solver trajectories exhibit task-preserving adaptation (Algorithm 1). These checks establish that the original strategy is invalidated while the task remains solvable. However, they do not formally guarantee that no secondary assumptions are affected or that every observed failure is attributable solely to the targeted assumption (more on this in our response to C5). We will clarify this limitation in the revised paper.

As acknowledged in Section 7, systematically studying multiple interdependent novelties is beyond our current scope. AGNI could be extended by introducing novelties sequentially and applying Algorithm 1's validation after each change. We leave empirical evaluation of this extension to future work.

AuthorsOpenReview ↗

C4: Generalization of Adaptation Improvements

C4. The reported gains in novel pass@1 are difficult to attribute to a genuine capability for diagnosing environmental changes and revising strategy, since both the training and evaluation novelties are constructed by the same GPT-5.5 analyzer over similar task distributions. The trained model may instead be acquiring shortcuts that memorize AGNI-style novelty patterns or produce meta-action labels as a formatting artifact, rather than learning general adaptation.

We agree that training and evaluation using the same AGNI pipeline could introduce shared novelty mechanisms. However, our experiments provide evidence that address both of your concerns:

(i) AGNI-specific shortcut learning: First, AGNI generates novelties based on assumptions underlying successful task-solving trajectories, rather than from a predefined set of perturbations. These assumptions depend on the tasks, environments, and agent strategies. Since our training and evaluation tasks are disjoint, the novelties implemented in the training and evaluation splits are also implicitly different. Despite this difference, novel pass@1 improves from 11.1% to 29.5% on ET-eval and from 2.7% to 5.0% on TB-Lite (Figure 5). This shows that training improves agents' ability to adapt to unseen tasks, environments, and the novelties introduced in them. Second, we evaluate models on paired base and novel tasks with unchanged prompt and graders. Since the novelty is not disclosed in the prompt, agents can only discover the environmental change through interaction and then revise their strategies to succeed, rather than simply replaying a memorized shortcut. Together, these observations suggest that training improvements extend to implicitly different novelties and improve agents' ability to adapt through interaction, rather than merely memorizing shortcuts.

(ii) Meta-action labels as formatting artifacts: We include controlled ablations in training-improvements to distinguish the effects of novelty-augmented training, META prompting, and META training (Section 6, Q6.2–Q6.3). First, novelty-augmented GRPO improves novel pass@1 from 11.1% to 29.5% without meta-action labels (Figure 5). Second, adding the META prompt during inference improves novel pass@1 from 29.46% to 32.59%, while training with META prompt further increases it to 37.86% (Table 3). These results demonstrate that META training provides additional gains beyond novelty-augmented training, rather than merely improving meta-action label formatting.

We acknowledge that we do not study generalization to independently constructed novelties that are explicitly different from those generated by AGNI. We leave this for future work and will clarify this limitation in the revised paper.

AuthorsOpenReview ↗

C5: Human Validation of Assumption Extraction and Novelty Alignment

C5. The pipeline is conditioned on the analyzer model's extraction of trajectory-relative assumptions, yet no precision estimate or error taxonomy is reported for this step, so if the analyzer systematically over-generalizes or misattributes assumptions the oracle check cannot detect the misalignment.

We agree that errors in assumption extraction could lead to misalignment between the extracted assumption and the actual implemented change. To evaluate this, we conducted a human study with 50 randomly sampled accepted AGNI task pairs. For each pair, the annotator examined the original task, successful base-task trajectories, extracted assumptions and their supporting evidence, and implemented environmental changes. We evaluated two criteria: (i) assumption validity, whether the extracted assumption is actually used by the agent in its successful trajectory, and (ii) novelty alignment, whether the environmental change actually targeted the assumption used by the agent. Each criterion was labeled Yes, No, or Unclear.

We found that 49/50 (98%) assumptions were valid, while 46/50 (92%) environmental changes targeted the identified assumptions. Of the 4 non-yes examples, 3 involved failures caused by changes affecting a different dependency than the selected assumption (for example, creating a file-path conflict by placing a non-empty directory at the file path rather than changing file permissions), while 1 was unclear. Overall, 46/50 (92%) task pairs satisfied both criteria, suggesting high assumption validity and novelty alignment among accepted AGNI task pairs.

This also highlights that AGNI's validation pipeline may not always ensure direct alignment between the extracted assumption and the implemented environmental change. Despite this, the validation checks in pipeline ensure that the novel tasks require agents to diagnose unexpected environmental changes and revise their strategies, making them useful for studying adaptation. These findings also provide empirical evidence relevant to C3. We will incorporate these findings and clarifications into the revised paper.

We hope our clarifications and additional empirical evidence have addressed your concerns. If so, we would appreciate it if you could reconsider your assessment and reflect any resolved concerns in your scores.

I thank the authors for their response, which addresses most of my concerns. I have raised my score.

Reviewer_KGVxOpenReview ↗
Rating
4
Confidence
3
Informativeness
2
Presentation
2
Soundness
3
Read review
Paper summary

Terminal agents increasingly run long tasks autonomously, and their strategies quietly depend on assumptions about the environment: nohup works, logs are UTF-8. Existing robustness benchmarks mostly use predefined perturbation families, which don’t fit open-ended terminal tasks, where what matters depends on the agent’s actual strategy. This paper introduces AGNI, a pipeline that starts from successful trajectories, extracts the assumptions they rely on, and breaks one of them while keeping the instruction, grader, and solvability fixed. Each novel task is checked so that the original oracle fails, an adapted oracle passes, and a solver can actually adapt without reward hacking.

Critical strengths
  • Strategy-relative novelty is the right framing for terminal agents. Breaking assumptions extracted from real trajectories is much more meaningful than a fixed perturbation list. The interact@1 check shows these novelties also hit models other than the one used to build them.
  • The validation pipeline is well designed. Each novel task must make the original oracle fail and an adapted oracle pass, must be solvable by a sampled solver, must show evidence of adaptation, and is rejected if any trajectory reward-hacks.
Critical weaknesses

GPT-5.5 is involved at every stage, including grading itself. The same model is the solver, analyzer, novelty generator, implementer, behavior validator, trajectory annotator, realism judge, and one of the evaluated models. A novel task is kept only if GPT-5.5 can solve it, so the eval set is selected for GPT-5.5 solvability, which plausibly flatters it. The stage labels behind the main mechanistic claims and all realism scores are GPT-5.5 judgments with no human audit or agreement numbers.

Questions for authors
  • Can you report a human audit of the adaptation-stage labels and realism scores, even on a small subset, and how much the results change if a different model replaces GPT-5.5 as the solver and judge?
2 comments
AuthorsOpenReview ↗

C1-C2: GPT-5.5 Construction Bias and Independent Validation

Thank you for your positive review of our work. We appreciate your recognition of strategy-relative novelty as the right framing for terminal agents and the strong design of our validation pipeline. We address your specific concerns below:

C1. GPT-5.5 is involved at every stage, including grading itself. The same model is the solver, analyzer, novelty generator, implementer, behavior validator, trajectory annotator, realism judge, and one of the evaluated models. A novel task is kept only if GPT-5.5 can solve it, so the eval set is selected for GPT-5.5 solvability, which plausibly flatters it. The stage labels behind the main mechanistic claims and all realism scores are GPT-5.5 judgments with no human audit or agreement numbers.

Thank you for raising this concern. We address it in detail in our response to C1 from Reviewer LYz2 and provide a brief summary below.

We first note that novel-task success is never judged by GPT-5.5. All novel tasks are graded by the original, unchanged deterministic graders. We agree that requiring GPT-5.5 to solve novel tasks may favor it, and its degradation is indeed generally smaller (Table 1). However, all seven models degrade substantially across three benchmarks, and novel-task interact@1 ranges from 90.7% to 99.0% across models. For adaptation-stage labels, re-annotating 600 trajectories with Sonnet-5.5 yields Cohen's kappa values of 0.878–0.912 across stages. Additionally, a human audit of 50 accepted task pairs found that 49/50 extracted assumptions were valid and 46/50 environmental changes aligned with the identified assumptions. Overall, these results suggest that such construction biases do not drive our main findings.

Dear reviewer, please respond to the author's comment to further facilitate the discussion as the author-reviewer discussion period ends at November 18 at 11:59pm AoE

Best, AC

Reviewer_LYz2OpenReview ↗
Rating
3
Confidence
3
Informativeness
2
Presentation
2
Soundness
3
Read review
Paper summary

The paper introduces AGNI, which modifies terminal environments while preserving task objectives and solvability. Across seven models and three benchmarks, these changes substantially reduce success rates. Novelty-aware training and explicit meta-action reasoning improve performance.

Critical strengths

Strong experimental design: paired environments, unchanged graders, solvability checks, and disclosure controls. Broad evaluation reveals meaningful differences between task competence and adaptation. Training experiments provide actionable findings, including limited benefits from process rewards.

Critical weaknesses

Potential construction bias: GPT-5.5 generates, filters, and judges the environments and trajectories. Independent audits would strengthen validity. Metric interpretation: The base–novel gap also reflects additional task difficulty and interaction cost, so it does not isolate adaptation ability. Limited transfer evidence: Held-out tasks still use AGNI-generated novelties; generalization to unseen failure mechanisms remains unclear. Uncertainty reporting: Missing confidence intervals and repeated training runs weaken conclusions about smaller gains, particularly paired training and META variants.

Questions for authors

Do the improvements persist on independently constructed novelties and under matched interaction budgets?

4 comments
AuthorsOpenReview ↗

C1: Addressing Potential GPT-5.5 Construction Biases

Thank you for your encouraging review and for raising several insightful questions. We appreciate your acknowledgment of our strong experimental design and actionable findings concerning adaptation in terminal agents. We address your specific concerns below:

C1. Potential construction bias: GPT-5.5 generates, filters, and judges the environments and trajectories. Independent audits would strengthen validity.

We agree that using GPT-5.5 throughout AGNI could introduce potential biases. We considered three major types of biases while designing AGNI: (i) generated novelties may disproportionately target only GPT-5.5's strategies, (ii) using GPT-5.5 as a solver may favor GPT-5.5's performance on novel tasks, and (iii) GPT-5.5-based annotations may introduce judgment bias, when evaluating its own trajectories.

Our experiments provide evidence that addresses these three potential sources of bias:

(i) Cross-model Relevance of Novelties: Although novelties are derived from GPT-5.5 trajectories, other models also interact with them frequently (Section 5, Q5.1). Novel-task interact@1 ranges from 90.7% to 99.0% across seven models, with GPT-5.5 generally achieving the highest interact@1. This suggests that novelties may be somewhat biased toward GPT-5.5's strategies, but their relevance extends broadly across models.

(ii) Selection Bias in Solver Performance: Requiring GPT-5.5 to solve novel tasks may favor its own absolute novel-task performance. However, we observe substantial performance degradation across all seven models and three benchmarks (Table 1), even though the degradation is generally smaller for GPT-5.5. This suggests that novelties may be easier for GPT-5.5, but the adaptation gap findings are not specific to GPT-5.5.

(iii) Judgment Bias in Trajectory: First, we observe similar adaptation-stage trends across different solver models, including DeepSeek-V4-Flash, while using GPT-5.5 as the trajectory analyzer (Figure 3b). Second, we independently annotated 600 randomly sampled GPT-5.5 solver trajectories using Sonnet-5.5, following the same annotation prompt as GPT-5.5. We treat each interaction turn as a classification instance, where each class (adaptation stage) can either be present or absent. We compute agreement between Sonnet-5.5 and GPT-5.5 as annotators and observe high cross-model agreement on adaptation-stage labels, with Cohen's kappa values of 0.912, 0.891, 0.878, and 0.901 for observe, recognize, diagnose, and revise, respectively. Overall, these observations suggest that our trajectory-level findings are unlikely to be driven by biases from GPT-5.5 evaluating its own trajectories.

Beyond these major biases, AGNI's validation pipeline provides additional safeguards for novel task construction. Each accepted novel task requires the original oracle solution to fail and the adapted solution to succeed, while task success is determined by unchanged, deterministic graders rather than LLM judgments. Furthermore, to independently audit task construction, we conducted a human study on 50 randomly sampled accepted task pairs (see our response C5 to Reviewer 4asx): 49/50 (98%) of the extracted assumptions were actually used in the successful trajectory, and 46/50 (92%) of the environmental changes targeted the identified assumption.

We acknowledge that using multiple models throughout the AGNI pipeline could further diversify generated novelties and help quantify model-dependent construction effects. However, a comprehensive cross-model construction study would require regenerating and validating environments, followed by downstream training and evaluation across models. This constitutes a substantial research study on its own, which we leave for future work.

We will incorporate these clarifications into the revised version of the paper.

AuthorsOpenReview ↗

C2–C4: Metric Interpretation, Generalization, and Training Uncertainty.

C2. Metric interpretation: The base-novel gap also reflects additional task difficulty and interaction cost, so it does not isolate adaptation ability.

We agree that the base-novel gap measures performance degradation under environmental novelty rather than isolating adaptation ability alone. Accordingly, throughout the paper, we interpret the adaptation gap alongside absolute base and novel success rates rather than relying on the gap alone (Section 3, L183–186).

Furthermore, our novelty-disclosed condition helps disentangle the sources of this degradation (Section 5, Q5.4). By explicitly disclosing the environmental change without providing a recovery strategy, we observe that 71.7% of the adaptation gap is recovered on average. This suggests that much of the degradation arises from the difficulty of diagnosing the novelty through interaction and revising the strategy, rather than solely from the increased difficulty of solving the task under the modified environment.

Finally, interaction budget is not a limiting factor. All models receive a maximum of 32 interaction turns (Appendix E.1) and novel trajectories average only 3–7 turns, just 0.8–2.2 turns more than base trajectories (Figure 3a). Weaker adapters (GPT-OSS-120B, Grok-4.20, Mistral-Large-3) use less than one additional turn on novel tasks and more often repeat failed strategies, despite substantial remaining budget (Section 5, Q5.5). Thus, the observed degradation is not simply due to insufficient interaction budgets.

Overall, our results provide evidence that the adaptation gap captures meaningful differences in adaptation ability, beyond the effects of increased task difficulty and interaction cost. We will emphasize these points more clearly in the revised version of the paper.

C3. Limited transfer evidence: Held-out tasks still use AGNI-generated novelties; generalization to unseen failure mechanisms remains unclear.

Our training and evaluation tasks are disjoint, and we additionally evaluate transfer from ET training to TB-Lite, a separate benchmark with characteristically different tasks (e.g., in terms of average interaction turns and task types). Importantly, AGNI generates novelties from assumptions underlying successful task-solving trajectories rather than sampling from a fixed set of perturbations. Since these assumptions depend on the underlying tasks, their environments, and the strategies used to solve them, novelties generated for TB-Lite are implicitly different from those generated for ET and need not follow the same distribution.

Our results show that novelty-augmented training improves novel-task performance on both ET-eval and TB-Lite. Figure 5 shows that novel pass@1 increases from 11.1% to 29.5% on ET-eval and from 2.7% to 5.0% on TB-Lite (Section 6, Q6.2).

We acknowledge that these results do not establish generalization to explicitly different, independently constructed novelties, which would require careful curation and retraining of models. We leave this for future work and will include this limitation in the revised paper.

C4. Uncertainty reporting: Missing confidence intervals and repeated training runs weaken conclusions about smaller gains, particularly paired training and META variants.

We agree that repeated training runs, larger evaluation sets, and confidence intervals would strengthen the interpretation of our training results. To quantify evaluation uncertainty, we compute two-sided 95% confidence intervals based on ET-eval rollouts.

Training methodNovel pass@1 (±95% margin)
Clean GRPO11.10 ± 1.84%
Novel-unpaired27.60 ± 2.62%
Novel-paired29.46 ± 2.67%
+ META Prompt32.59 ± 2.75%
+ META Training37.86 ± 2.84%
+ Recovery & Verify38.00 ± 2.84%
+ Diagnosed Exploration25.14 ± 2.54%
+ Exploration & Completion38.80 ± 2.85%

These results support our two main conclusions: (i) novelty-augmented training produces statistically significant improvements over clean GRPO (11.10% to 29.46%), and (ii) META training further significantly improves performance over both novel-paired GRPO (29.46% to 37.86%) and META prompting (32.59% to 37.86%). In contrast, the smaller positive improvements from paired versus unpaired training and process-reward variants are not statistically significant under the current evaluation.

We acknowledge that repeated training runs and larger evaluation sets would provide additional evidence about the reliability of these improvements, particularly the smaller differences between training variants. We will clarify this limitation in the revised paper.

AuthorsOpenReview ↗

C5: Clarifications on Generalization and Interaction Budgets

C5. Do the improvements persist on independently constructed novelties and under matched interaction budgets?

As discussed in C2 and C3, our current experiments address these concerns. Transfer to TB-Lite suggests that training improvements extend to implicitly different novelties arising from different tasks and environments. Similarly, interaction budget is not a limiting factor: novel trajectories average only 3-7 of the 32 available turns, and improvements under the novelty-disclosed condition suggest that performance degradation is not solely attributable to interaction cost but also to difficulties in diagnosing novelty and revising strategies. We agree that evaluation on independently constructed novelties will further provide stronger evidence for generalization. We will clarify these limitations in the revised paper.

We hope our clarifications and additional empirical evidence have addressed your concerns. If so, we would appreciate it if you could reconsider your assessment and reflect any resolved concerns in your scores.

Dear reviewer, please respond to the author's comment to further facilitate the discussion as the author-reviewer discussion period ends at November 18 at 11:59pm AoE

Best, AC

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

Related papers

Loading the map…

Discussion (0)

Sign in to comment.