acceptodds
Under review as a conference paper at ICLR 2027

Beyond Current-Task Success: Revision Sufficiency for Learning Agents

Abstract

Agents compress experience into reusable strategies for the objective at hand. A strategy that improves current execution may nevertheless become inadequate when the success criterion changes. We study *revision sufficiency*: whether a retained representation supports behavior under a specified revised criterion, without additional adaptation episodes before held-out evaluation. On procedurally generated tool-use tasks, we compare a trajectory archive with a strategy built from the same evidence for the original objective. Planning and execution are matched across representations within each stage. In a preregistered study of seeds with complete pairs, the strategy succeeds more often before revision ( versus ) but percentage points less often afterward. A separate control constructs the strategy for the revised objective under the same length cap; it then outperforms both the original-objective strategy and the archive after revision. These results distinguish the immediate usefulness of goal-specific preprocessing from the ability to reuse experience under a changed objective. Current-task acceptance can favor the former without establishing the latter. This paper identifies an overlooked factor in long-running self-evolving agent systems.

Primary area:
datasets and benchmarks
Keywords:
context engineering, self evolve agent

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.00 over 3 reviews, above 0% of the others.
Reviewer_yZrpOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper introduces “revision sufficiency,” asking whether experience retained for an original objective remains useful after the success criterion changes. The authors compare a trajectory archive with a compact strategy constructed from the same experience for the original objective. In a synthetic tool-use environment, the original objective checks two directly updated variables, whereas the revised objective additionally requires a variable governed by a hidden ordering constraint. On 507 complete paired seeds, the compact strategy performs better before revision but substantially worse afterward. A separate control shows that constructing the strategy for the revised objective under the same length cap improves revised-task performance. The paper also presents execution audits, additional controls, and a proposed evidence-dependency framework called LEDGER.

Critical strengths
  1. The paper raises a relevant concern for agents that convert experience into reusable strategies: improvement on the current objective does not establish usefulness under future requirements.

  2. The primary comparison uses the same source experience and matches planning and execution conditions within each stage. The revised-objective builder control is useful because it distinguishes the construction objective from the length cap. Additional controls holding the instance and budget fixed strengthen the interpretation of the behavioral result.

  3. The authors transparently report protocol limitations, unsuccessful diagnostics, and negative results. Sensitivity analyses show that missing outcomes and the undeclared turn guard cannot fully explain the direction of the post-revision difference. A fixed-representation second-reader experiment also reproduces the ranking reversal, although with a smaller effect.

Critical weaknesses
  1. Limited novelty. The central finding is a relatively predictable limitation of objective-specific lossy compression: information unnecessary for the original objective may become necessary later. The paper does not sufficiently establish what “revision sufficiency” adds beyond this observation.

  2. Narrow empirical scope. The main evidence comes from one synthetic task family, one objective expansion, and a very small archive. The second-reader experiment reproduces the reversal, but realistic workloads, cross-structure transfer, and repeated revisions remain unestablished. Hundreds of seeds improve within-task precision rather than external validity.

  3. Unresolved mechanism. Text-matching audits cannot distinguish information loss from utilization difficulty. Evidence add-back does not establish behavioral recovery, archive interventions do not localize the effect, and the gradient diagnostic fails qualification. The paper establishes the behavioral gap more clearly than its cause.

  4. Unvalidated practical recommendations. LEDGER remains a design proposal, while scope stamps and archive pointers are untested. The small archive also leaves the practical tradeoff between compression, evidence retention, and retrieval cost unresolved. Table 1 partly emphasizes corrected evaluations, whereas the main experiment tests objective expansion.

  5. Protocol and statistical limitations. The undeclared turn guard affects the two paths unequally; sensitivity bounds protect the direction but not the effect size under the intended budget. The preregistered gates do not directly establish ranking reversal, which instead relies on separate paired contrasts.

Questions for authors
  1. What specific conceptual or empirical finding distinguishes revision sufficiency from the expected limitations of representations constructed for an earlier objective?

  2. Does the main result persist when unsuccessful combination returns an explicit error, the preparation state is observable, or different variables become relevant after revision?

  3. How does the archive compare with compact representations explicitly designed to preserve operation rules, failure conditions, and evaluation scope without knowing the specific future objective?

  4. What evidence supports applying the findings to repeated strategy updates in realistic agent systems, beyond the isolated handoff evaluated here?

  5. Can the authors provide anonymous, timestamped registration and amendment records and clearly separate registered analyses from exploratory ones?

Reviewer_LiCCOpenReview ↗
Rating
1
Confidence
4
Informativeness
1
Presentation
1
Soundness
2
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Paper summary

The paper studies whether experience organized for a current objective remains useful after that objective changes, and proposes revision sufficiency as an evaluation criterion. To test this under controlled conditions, the authors build an environment with procedurally generated tool-use tasks. They compare the original interaction records (the archive) with a short strategy written from those records for the original task. The revision expands the success criterion from two state variables to three. Of 600 assigned source seeds, 507 yield complete paired results. Before revision, the strategy achieves 99.2% success, compared with 89.2% for the archive. After revision, these rates become 5.3% and 53.1%. A control that rebuilds the strategy for the revised objective shows that the same word limit can support substantially better post-revision performance. The paper also examines the result through controls that fix the instance and budget, a second reader model, and execution-trace analysis. A strategy that helps an agent solve the original task may fail when the task requirements change. The authors suggest keeping the original records so that a new strategy can be built for the revised task.

Critical strengths
  1. The two representations are built from the same source records, and the paper includes controls that fix the instance and execution budget. The paired design and sensitivity analyses support the reported ranking reversal. The main behavioral result is credible within the tested setting.

  2. A strategy built for the revised objective recovers good performance under the same word limit. This helps rule out insufficient text length as the sole explanation for the failure.

Critical weaknesses

Weakness1: The experimental scope is narrow, and the dependence of the findings on the particular task construction remains untested.

The main experiment uses one task mechanism and one type of objective revision: the original objective checks two directly updated variables, and the revision adds a third variable that requires a specific sequence of calls. Changing tool names, variable names, and constants produces more instances of the same problem. Table 14 explores changes to task structure and operation rules, but compares the archive with no experience. The new-structure conditions are near the floor, and the changed-rule result is inconclusive. These comparisons do not establish whether the ranking reversal between the old strategy and the archive persists under different task mechanisms.

The archive is constructed to contain the rule needed for the revised objective, while the old strategy is generated for an objective that does not require that rule. Hidden state, silent ineffective calls, queries that cancel preparation, and a limited execution budget make rediscovering the rule difficult. Together, these choices make failure of the old strategy fairly predictable. The paper does not show how much of the archive's advantage remains when these conditions are relaxed. More seeds improve the precision of the estimate within this setting, but cannot address the lack of diversity in task mechanisms and objective revisions.

The analysis also does not distinguish information omitted from the strategy, information retained but not used by the planner, and failures during worker execution. Text matching alone cannot establish information loss. The evidence add-back experiment in Appendix J completed only six of the 16 registered seeds and has not established clear behavioral recovery. Appendix H.2 compares rewriting the old strategy with rebuilding from the archive. The latter works better in the tested task, but the case for retaining source records under other task mechanisms or objective revisions remains unresolved.

I would prioritize separate tests in which ineffective operations return explicit errors and queries no longer cancel preparation, holding the other settings fixed and reporting whether the gap shrinks or disappears. These ablations are listed in Appendix Q.1 but have not been run. Targeted evidence add-back could also help determine which omissions contribute to behavioral failure.

The study provides limited insight into which objective revisions cause failure, when they do not, or how to anticipate and mitigate that failure. This is the main reason for my rejection recommendation. I would reconsider with evidence that tests the dependence on the conditions above or validates the finding in a different task mechanism or type of objective revision. Additional instances or seeds, more detailed statistical reporting, or presentation changes alone would not resolve this concern.

Weakness2: The task description and organization make the paper difficult to follow.

Understanding what the experiments compare and which conclusions they support requires repeatedly consulting the main text, figures, and appendices. The task is still unclear when factual sufficiency, behavioral sufficiency, revision sufficiency, and the multistage protocol are introduced. Readers must work out the relationship between source and evaluation instances, distinguish the stored strategy from the guidance generated at execution time, and track changes in both objectives and instances. The introduction focuses on long-term self-evolving agents, while the main experiment tests a single controlled handoff of experience. Substantial space devoted to diagnostics and unevaluated system designs further obscures the main contribution.

Figures 3 and 4 place important experimental conditions and analysis details in small, low-contrast text. Figure 6 is rotated and densely packed. The main evidence, supporting diagnostics, and untested designs are spread across several appendices, making it difficult to check the basis for each claim.

A worked example would help: show the original records and old strategy, explain what the revised objective adds, and compare the resulting guidance and execution. The paper should also distinguish its main empirical findings from supporting diagnostics and future designs. Figures should contain only the necessary labels, with full experimental conditions in readable captions or tables.

Questions for authors
  1. Does the performance gap between the archive and the old strategy persist when ineffective operations return explicit errors, or when queries no longer cancel preparation? Do you have experimental results for either change?

  2. How does the existing evidence distinguish information lost from the strategy, information not used by the planner, and worker execution failures? What conclusions are supported by the completed evidence add-back experiments in Appendix J?

Reviewer_gfb6OpenReview ↗
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1
Confidence
2
Informativeness
1
Presentation
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Soundness
1
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Paper summary

The paper investigates revision sufficiency--whether an agent’s strategy, summarized from past experience for one goal, remains useful when the goal changes.

Suppose there are two agent tasks, A and A', that are almost identical except for their success criteria: A' has one additional requirement. An agent is asked to reflect on experience from A and save a strategy Cg0C_{g_0} in memory. On A', performance when using Cg0C_{g_0} is worse than when using the original trajectory archive TT. The paper studies this as a failure of revision sufficiency.

The paper empirically demonstrates that this problem exists in a synthetically generated tool-use task. The main result is in Figure 3(a): using Cg0C_{g_0} outperforms using TT on the original task A, but underperforms it on the variant task A'.

Additional experiments vary the tool-call budget, change the historical success/failure labels, and modify how the archive TT is generated.

Critical strengths
  • The paper finds that agent reflection can lead to “overfitting” to the current success criterion and worse generalization to new task variants. This finding could be useful to some readers.
  • Clean diagrams and visualizations.
Critical weaknesses
  • The paper is extremely difficult to read. In my view, the central issue is a drop in test performance under an objective shift (a form of distribution shift). Coining the term “revision sufficiency” adds to the reader’s cognitive load without making its distinct contribution clear. Other unnecessary jargon includes “announcement,” “source briefing,” and “behavioral sufficiency.”

  • The experimental setup is very difficult to understand.

    • Dataset: The paper introduces a new procedurally generated tool-use task, but provides insufficient concrete detail. At a minimum, the paper should include the available actions and their argument schemas, along with one complete task example.
    • Models: All models and their roles should be introduced together, ideally in an experimental setup section. The paper uses ds-v4.1-flash, gemma-4-E2B-it, and MiniMax-M3, but introduces them in a scattered manner.
  • Beyond the synthetic task family, for which concrete examples are lacking, the paper could be strengthened by experiments on at least one realistic agent benchmark.

Questions for authors
  • Can you provide concrete examples of Cg0C_{g_0} and Cg1C_{g_1}?
  • Did you use an open-source agent harness or develop your own for the experiments?
  • Can you further elaborate on the significance of the finding? For example, what risks does it pose to realistic long-running agents?

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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