acceptodds
Under review as a conference paper at ICLR 2027

Not All Thoughts Are Worth Thinking: Reliability-Aware Test-Time Scaling

21 views

Abstract

Test-time scaling improves LLM reasoning, but concept-guided inference can waste compute on weak or redundant solving directions. We study pre-expansion concept allocation: which explored concepts should receive solution-generation compute? We introduce RATTS, a Reliability-Aware Test-Time Scaling method that combines calibrated predictions of judged concept usefulness with semantic soft coverage. Its objective favors useful, complementary concepts, is monotone submodular, and admits a greedy approximation guarantee; under an explicit concept-success model, we further derive a conditional bound connecting the surrogate to candidate recall. Across Math500, GPQA Diamond, and HumanEval+ with three generators, RATTS achieves macro-average pass-any at and , versus for score-only selection and for uniform-weight semantic coverage. RATTS retains of full-expansion pass-any while reducing exploration-plus-expansion tokens by . Macro-average final accuracy is versus for full expansion, with a paired difference of pp ( CI: ). To enable reproduction of these results, we will release the code and experimental artifacts upon acceptance.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Test-Time Scaling, LLM Reasoning, Inference-Time Compute, Submodular Optimization, Compute-Efficient Inference

Reviews

Among:
Shape:
1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_ZQMFOpenReview ↗
Rating
2
Confidence
3
Informativeness
1
Presentation
2
Soundness
1
Read review
Paper summary

This paper studies pre-expansion concept allocation in concept-guided test-time scaling. Concept-guided inference first generates a pool of high-level concepts, and the key question is which of them should receive solution-generation compute before any rollout outcome is observed. The proposed method (RATTS) scores each concept with a lightweight relevance model (BGE-small) trained on LLM-judge usefulness labels which measures overlap between concepts with embedding similarity. It then selects a fixed fraction of concepts by greedily maximizing a relevance-weighted soft-coverage objective.

Critical strengths

The paper has clear problem and methodology framing, with comprehensive evaluation. The paper compares selectors on identical concept pools and stored rollouts through offline replay, which isolates the allocation decision.

Critical weaknesses
  1. The methodological novelty is limited and incremental. Each part of RATTS is a well-known technique added to the two-stage setup (propose concepts, then expand them into solutions) comes directly from GuidedSampling. The authors themselves say (Appendix A) that the selection algorithm is not the contribution, and that the novelty lies in framing the problem and connecting their objective to candidate recall. That connection adds little. Proposition 3.1 shows that the chance of at least one success can only grow, with diminishing returns, as more concepts are added. That is close to obvious. Theorem 3.3 first assumes a model under which recall takes exactly the same form as their objective, then bounds the gap when the parameters differ. The conclusion is largely built into the assumption. The authors also admit the actual scorer may not satisfy this model, so the guarantee does not clearly apply to the method as used. Overall, the paper applies a standard relevance-plus-diversity selection method to a new setting rather than proposing a new method.

  2. The gain is small compared to training-free baselines. The gain over simple baselines is small. At the main setting (Table 5), RATTS reaches 95.65% pass-any. Simple selectors that need no training come close: Random Cluster gets 94.61%, Top Cluster Representatives 94.53%, MMR 94.55%, and uniform soft coverage 94.45%. The strongest PRM baseline, ReasonFlux (95.12%), is not significantly different. The results therefore show mainly that skipping near-duplicate concepts helps, which almost any diversity-aware method achieves. They do not show that RATTS in particular is needed. Final accuracy is about the same as expanding every concept (74.42% vs. 74.08%, CI [−0.90, 1.62]), and drops by 5.5 points on HumanEval+ with GLM-4.7-Flash. The paper reports no final-accuracy comparison against Random Cluster or MMR, so we cannot tell whether the recall gain improves the answers.

  3. The cost is not justified. RATTS adds costs that the baselines avoid that are not counted. To get the marginal gain, RATTS needs a separate scorer for each generator where each scorer is trained on 2.9k–7.6k concepts labeled by GPT-5.5 Pro with extended reasoning, and extra steps for calibration and checkpoint selection. None of the labeling or training cost appears in the token accounting. At inference time, RATTS is also slower than Random Cluster.

Questions for authors
  1. Can you report final-answer accuracy, not only pass-any, for Random Cluster, MMR and uniform soft coverage at matched budgets? Does RATTS’s ~1-point recall gain over these baselines carry through to final accuracy?

  2. What is the total cost of building each generator-specific scorer: the number of GPT-5.5 Pro judge calls, tokens, and the training and calibration compute? At what deployment volume does it pay off compared with a training-free selector such as Random Cluster or MMR?

  3. How sensitive is RATTS to the choice of judge? Would labels from a weaker, open-weight judge, or labels derived from rollout outcomes, give similar gains? Can one scorer transfer across generators without retraining?

  4. Across the full ρ\rho sweep, and especially at small budgets (ρ≤0.2\rho\leq0.2) where selection matters most, how does RATTS compare with Random Cluster and MMR? Is the gap larger than at ρ=0.3\rho=0.3?

4 comments
AuthorsOpenReview ↗

Response to the Reviewer ZQMF

Thank you so much for your time and constructive feedback to improve the paper. Below, we address all your concerns.

Regarding the Novelty.

Our contribution is to formulate concept expansion as a budgeted selection problem and analyze its connection to candidate recall. We agree that Proposition 3.1 has a straightforward proof. However, its role is to establish that diminishing returns are a property of actual candidate recall, even when concept successes are dependent. This provides a structural property for the selection objective to preserve, without establishing that any particular surrogate approximates the recall well. Proposition 3.2 then addresses a different, but important practical question by giving a computable upper bound on how much the optimal allocation could improve coverage at the same budget.

Regarding Theorem 3.3, the success-mode assumption supplies the ideal model under which recall has the product form. The additional result is a lower bound relative to optimal concept selection when the implemented weights and similarities differ from the model probabilities. The bound accounts separately for these errors and shows how the similarity-error contribution grows with the selection budget. Thus, the analysis distinguishes the loss from subset optimization from the error introduced by approximating recall with coverage. Its practical value is to identify what must hold for the coverage guarantee to extend to recall and how imperfect estimates weaken that guarantee.

In the revised version, we also added an empirical check using actual correctness outcomes from stored rollouts. Across 2.28 million equal-budget subsets, the upper coverage quartile achieves 0.233 percentage points higher candidate retention than the lower quartile. This supports a positive relationship between the implemented objective and candidate retention (Appendix D.6, "Coverage and retained candidate recall"). This supports the conditional analysis without establishing that the model assumptions hold or estimating its approximation errors.

Regarding the Gains over Simpler Selectors.

The gains also extend to final-answer accuracy. At the same expansion budget, RATTS achieves observed macro-average gains of 5.16 percentage points over Random Cluster, 1.93 over MMR, and 2.69 over uniform coverage. The table below reports both pass-any and final-answer accuracy at K_max = 50 and ρ = 0.30.

MethodPass-any (%)Final-answer accuracy (%)
RATTS95.6574.42
Random Cluster94.6169.26
MMR94.5572.49
Uniform coverage94.4571.73

These comparisons were already reported in Appendix D.6. In the revised version, we also compare pretrained PRM weights within the same coverage selector. We observe that RATTS achieves 74.42% final-answer accuracy, compared with 73.45% for SkyWork-weighted coverage and 73.23% for ReasonFlux-weighted coverage. This comparison tests the choice of scorer while keeping the coverage objective and expansion budget fixed. Note that the RATTS scorer has approximately 33M parameters, compared with 1.5B parameters for each evaluated PRM.

Further, compared with full expansion, the main benefit is efficiency. RATTS reduces exploration-plus-expansion tokens by 56.69%, with observed macro-average final-answer accuracy of 74.42% versus 74.08%. As rightly observed, final accuracy is higher in seven settings, equal in one, and lower in one. The exception is HumanEval+ with GLM-4.7-Flash, where accuracy decreases from 77.44% to 71.95%. This programming benchmark is outside the scorer's training domain of mathematical concept judgments and hence acts as an out-of-distribution task.

AuthorsOpenReview ↗

Response to the Reviewer ZQMF [Continued]

Regarding Scorer Preparation and Cost.

The scorer is trained once and then reused, so labeling and training are a one-time cost per generator. Further, in the table below, we report the recorded concept-generation tokens and training times for each scorer.

GeneratorGenerated tokensTraining time
Qwen3.5-9B193,4738 min 18 sec
Gemma4-E4B3,070,72715 min 55 sec
GLM-4.7-Flash565,14111 min 58 sec

As shown in the table, generating the training concepts across all three generators produced approximately 3.83 million tokens. This preparation cost is incurred once and shared across subsequent inference requests. For illustration, the same output-token volume would cost less than 50 dollars at GPT-6.1 Sol's standard rate. Regarding the judge cost, unfortunately, we did not log the judge-token usage and do not have a verified judge-call count. However, labeling all the concepts across the three generators took less than 15 minutes in total.

Next, Table 18 of the revised paper also shows that a scorer can be reused across the evaluated generators without retraining or recalibration, with similar observed macro-average accuracy. Our MMR baseline uses the same learned scorer and therefore shares its preparation cost.

Compared with scorer-free uniform coverage, RATTS adds 48.33 ms of median selection time per question. In the recorded end-to-end measurement, the mean increase is just 0.26 seconds per question, which is approximately 0.08% of the uniform-coverage latency. These increases accompany observed gains of 2.69 percentage points in final-answer accuracy and 1.20 percentage points in pass-any, without increasing the expansion budget. RATTS also achieves 74.42% final-answer accuracy compared with 69.26% for Random Cluster, an observed gain of 5.16 percentage points at the same expansion budget. Thus, the benefit of the additional selection computation extends to the accuracy of the returned answers.

Regarding Judge Choice and Scorer Transfer.

RATTS uses supervised learning, so its performance depends on the quality of the training labels. If a weaker judge provides poorer or misleading labels, these can affect the scorer's performance. Labels derived from actual rollout outcomes, however, would provide direct supervision on expansion success and give the best performance, but generating these labels is computationally costly. This is why we use proxy labels provided by a judge.

Further, we also evaluate whether a scorer can transfer across generators without retraining or recalibration. The table below reports macro averages across the same nine dataset–generator settings. Using a single scorer across all three generators gives observed final-answer accuracy between 74.33% and 74.60%, compared with 74.42% when using a matching scorer for each generator. These results support reusing a scorer across the evaluated generators and sharing its preparation cost. This comparison is reported in Appendix D.6 under "Cross-generator scorer transfer" (Table 18).

Scorer used for selectionPass-any (%)Final-answer accuracy (%)
Matching scorer for each generator95.6574.42
Qwen-trained scorer on all generators95.6874.60
Gemma-trained scorer on all generators95.4774.45
GLM-trained scorer on all generators95.8274.33
AuthorsOpenReview ↗

Response to the Reviewer ZQMF [Continued]

Regarding Comparisons Across Expansion Budgets.

We have added comparisons with MMR and Random Cluster for expansion fractions from ρ = 0.10 to ρ = 0.50. As shown in the table below, RATTS achieves higher observed pass-any and final-answer accuracy than both methods at every budget in this range. These results are also reported in Appendix D.3, Table 12.

ρRATTS pass-any (%)MMR pass-any (%)Random Cluster pass-any (%)RATTS final accuracy (%)MMR final accuracy (%)Random Cluster final accuracy (%)
0.1092.5991.8089.6671.9771.2365.33
0.1594.0493.2392.0973.1972.8666.67
0.2094.6893.8692.9973.3472.0267.14
0.2595.2894.1894.1574.2072.2367.89
0.3095.6594.5594.6174.4272.4969.26
0.3595.8494.7795.1774.2072.3068.99
0.4095.9794.8495.5174.6772.4469.26
0.4596.1395.2195.6574.6272.5669.57
0.5096.1595.2195.7574.8272.3469.94

The gap over Random Cluster is indeed larger at the smallest evaluated budget. At ρ = 0.10, RATTS improves pass-any by 2.93 percentage points and final-answer accuracy by 6.64 points, compared with 1.04 and 5.16 points at ρ = 0.30. This shows that the benefit over Random Cluster is particularly clear when only a small fraction of the concepts can be expanded.

For MMR, RATTS also has higher observed accuracy throughout the reported range, although the gap is not consistently larger at smaller budgets. At ρ = 0.10, the gains are 0.79 percentage points in pass-any and 0.74 points in final-answer accuracy, compared with 1.10 and 1.93 points at ρ = 0.30.

AuthorsOpenReview ↗

Follow-up on the Rebuttal

Dear Reviewer ZQMF,

Thank you again for your review. We believe that our response addresses the concerns raised in your review. As the discussion period is approaching its end, we would appreciate it if you could take a look and let us know if any concerns remain or if any further clarification would be helpful.

Best regards,

The Authors

Reviewer_YXJLOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper studies pre-expansion concept allocation for test-time scaling: given a pool of high-level solving concepts, it selects a budgeted subset before generating concept-conditioned solutions. The proposed RATTS method combines a lightweight predictor trained on LLM-judged concept usefulness with semantic similarities through a weighted soft-coverage objective, optimized greedily. The paper establishes submodularity properties and a conditional connection between the surrogate and retained candidate recall. Experiments use shared-pool offline replay across three benchmarks and three generators, reporting candidate recall, final-answer accuracy, generation-token costs, and selector latency. RATTS retains most of the candidate recall of full expansion while reducing generation costs, although several final-answer comparisons remain statistically unresolved.

Critical strengths

The reported generation savings are substantial: RATTS reduces exploration-and-expansion tokens by 56.69% while retaining 98.7% of the full-expansion pass-any rate. The comparison with uniform-weight coverage also helps assess the contribution of learned usefulness weights.

Critical weaknesses
  • Limited methodological novelty. The method combines a concept-level usefulness scorer, analogous in role to a PRM, with standard probabilistic coverage [3]. Selecting concepts before generation is a distinction, but the paper lacks experimental comparisons with closely related methods, including REBASE [1] and DORA [2].

  • Insufficient evidence for the added scorer’s practical value. Evaluation is limited to three established benchmarks: MATH500, GPQA Diamond, and HumanEval+. The 1.20 percentage-point pass-any gain over uniform coverage has a positive reported confidence interval, but the final-accuracy difference is not statistically resolved (Appendix D.6). Robustness across independent scorer training and fresh generation pools is untested. Moreover, existing PRM scores are not compared using the same coverage selector, leaving the need for a separately trained scorer insufficiently justified.

[1] Inference Scaling Laws: An Empirical Analysis of Compute-Optimal Inference for LLM Problem-Solving. ICLR 2025.

[2] Every Rollout Counts: Optimal Resource Allocation for Efficient Test-Time Scaling. NeurIPS 2025.

[3] Turning Down the Noise in the Blogosphere. KDD 2009.

Questions for authors
  • Positioning and comparison: What specific allocation capability does RATTS add beyond REBASE [1] and DORA [2]? Please distinguish the pre-expansion concept-subset formulation from prior allocation over partial trajectories, and provide a controlled comparison or explain the methodological obstacles to a meaningful comparison. A comparison should make any adaptations and total inference-cost accounting explicit.

  • Validity of the surrogate: Is there empirical evidence that the judged-usefulness scores predict actual expansion success, and that semantic similarities reflect overlap in successful expansions? Theorem 3.3 is explicitly conditional, but the current diagnostics concern agreement with judge labels rather than the success quantities appearing in that theorem. Evidence from the stored rollouts could materially clarify the significance of this connection.

  • Practical contribution: Do final-answer accuracy versus total inference-cost comparisons among RATTS, uniform coverage, MMR, and existing PRM scores combined with the same coverage objective demonstrate a consistent advantage for the learned usefulness component? The current operating-point and independent-ranking comparisons do not fully resolve this question.

[1] Inference Scaling Laws: An Empirical Analysis of Compute-Optimal Inference for LLM Problem-Solving. ICLR 2025.

[2] Every Rollout Counts: Optimal Resource Allocation for Efficient Test-Time Scaling. NeurIPS 2025.

3 comments
AuthorsOpenReview ↗

Response to the Reviewer YXJL

We thank the reviewer for their constructive comments and for suggesting additional baselines. These suggestions helped us clarify the contribution and strengthen the evaluation.

Regarding the Novelty and Comparison with Prior Methods.

As clarified in Appendix A, our contribution is to formulate concept allocation before solution generation and analyze its connection to candidate recall. RATTS decides which concepts to expand before generating any partial solutions. REBASE and DORA allocate continuations among partially generated solutions. A direct comparison requires fresh adaptive generation so that REBASE and DORA can request new continuations as they run. Such a comparison should use the same base generators and match the total inference budget, including generation, reward scoring, similarity computation, and selection. Appendix A now explains these requirements for a controlled comparison.

Further, for this concept allocation problem, Proposition 3.2 gives a computable upper bound on how much an optimal subset could improve coverage at the same budget. Under the stated assumptions, Theorem 3.3 gives a lower bound on the candidate recall retained by RATTS relative to the best subset at the same budget, accounting for errors in the weights and similarities. These bounds tell us how much room there is to improve coverage and how much candidate recall RATTS is guaranteed to retain under those assumptions.

We also examined the relationship between coverage and candidate retention empirically in Appendix D.6 under "Coverage and retained candidate recall." Comparing subsets of the same size within each problem, we found that higher-coverage subsets had a retention rate 0.233 percentage points higher than that of lower-coverage subsets. This supports a positive relationship between coverage and candidate retention in the evaluated pools.

About Insufficient Evidence and Practical Value of the Scorer

We intentionally chose these datasets, as they cover three different settings. In Math500, the dataset is completely in-distribution with S1K; in GPQA, it is partially; and in HumanEval+, it is totally out of distribution with the training data. Further, thanks for the interesting baseline on PRM with the same coverage, which we somehow missed. We have these results in Appendix D.6 under "Accuracy with pretrained PRM weights" (Table 17), which shows that RATTS achieves 74.42% observed macro-average final-answer accuracy, compared with 73.45% for SkyWork-weighted coverage and 73.23% for ReasonFlux-weighted coverage. Note that our scorer has approximately 33M parameters, compared with 1.5B for each evaluated PRM. Table 18 additionally reports similar observed accuracy when reusing a scorer across generators without retraining or recalibration. This tests cross-generator reuse.

We further check whether higher usefulness scores lead to better solution outcomes using the stored rollouts. As observed, the upper usefulness-score quartile achieves 74.11% final-answer accuracy, compared with 71.79% for the lower quartile, an observed improvement of 2.32 percentage points. Similarly, the difference in the pass-any accuracy is around 0.279 percentage points. The final-answer comparison therefore provides additional evidence about the value of score-based selection.

To examine the coverage–recall connection in Theorem 3.3, we also test coverage against actual solution outcomes using the stored rollouts. Across 2.28 million subsets, we compare subsets of the same size within each problem and measure whether their solutions contain at least one correct answer. The upper coverage quartile achieves 0.233 percentage points higher retention than the lower quartile. Thus, at the same expansion budget, higher coverage is associated with a greater chance of retaining a correct solution. This provides empirical evidence about the surrogate's connection to candidate recall beyond agreement with judge labels, as reported in Appendix D.6 under "Coverage and retained candidate recall", and complements the theorem's conditional guarantee, without estimating its approximation errors.

AuthorsOpenReview ↗

Response to the Reviewer YXJL [Continued]

Regarding Practical Contribution

The table below compares final-answer accuracy and generation cost at K_max = 50 and ρ = 0.30. The values are equal-weight averages across the nine dataset–generator settings. As seen, RATTS achieves observed gains of 2.69 percentage points over uniform weights, 0.97 over SkyWork, and 1.19 over ReasonFlux. The 1.93-point gain over MMR compares the selection rules using the same learned scores and similarities. Also note that SkyWork and ReasonFlux are 1.5B models, compared with the 33M-parameter RATTS scorer.

MethodFinal-answer accuracy (%)Generation tokens per question
RATTS (33M)74.42142,709.8
Uniform coverage71.73142,828.9
MMR72.49—
SkyWork PRM (1.5B) + coverage73.45142,479.6
ReasonFlux PRM (1.5B) + coverage73.23142,584.4

These observed accuracy gains come with essentially unchanged generation-token usage. Compared with uniform coverage, RATTS adds 48.33 ms of median selection time per question. Further, in the end-to-end measurement, the observed increase in mean latency is just 0.26 seconds per question, approximately 0.08% of the uniform-coverage latency. Thus, the observed improvement in final-answer accuracy comes without increasing the expansion budget and with very little additional end-to-end time in this measurement. Further details are provided in Appendix D.6 under "Accuracy and computational cost of learned weighting" and "Accuracy with pretrained PRM weights".

AuthorsOpenReview ↗

Follow-up on the Rebuttal

Dear Reviewer YXJL,

Thank you again for your review. We believe that our response addresses the concerns raised in your review. As the discussion period is approaching its end, we would appreciate it if you could take a look and let us know if any concerns remain or if any further clarification would be helpful.

Best regards,

The Authors

Reviewer_JvLPOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper proposes Reliability-Aware Test-Time Scaling (RATTS), a framework for selecting promising and complementary reasoning concepts before allocating computation to full solution generation. RATTS combines a learned concept-usefulness scorer, calibrated using LLM-generated judgments, with a relevance-weighted semantic coverage objective. The authors show that the proposed surrogate is monotone submodular and admits a greedy approximation guarantee, and further derive a conditional connection to candidate recall under an explicit success-mode assumption. Experiments across three benchmarks and three language models demonstrate that RATTS preserves most of the candidate recall achieved by full concept expansion while substantially reducing generation costs.

Critical strengths

The paper addresses the computational inefficiency of expanding redundant or unpromising reasoning concepts. The proposed formulation of concept allocation as a budgeted subset-selection problem is reasonable and provides a structured perspective on inference-time computation allocation.

Critical weaknesses
  1. My primary concern is that the core methodological contribution is relatively incremental. The proposed framework combines a learned relevance score with a semantic coverage objective, which is closely related to established relevance–diversity subset-selection methods. The monotone submodularity and greedy approximation guarantee follow from the chosen coverage formulation, rather than representing a fundamentally new optimization principle.

  2. The theoretical analysis is presented as an important contribution, but its practical implications are limited. The greedy approximation guarantee establishes near-optimality with respect to the constructed surrogate objective, not the actual probability of generating a correct solution. The connection to retained candidate recall in Theorem 3.3 further depends on a restrictive success-mode assumption and the approximation errors between the surrogate parameters and the underlying concept-success probabilities. In particular, the practical relevance weights are derived from LLM-judged usefulness, while semantic similarities are computed using cosine similarity between text embeddings. Neither quantity is explicitly trained to estimate the latent success-mode probabilities required by the theoretical model. The paper does not empirically quantify these approximation errors or establish that the resulting bound is informative in the evaluated settings. Consequently, the theoretical results provide limited justification for why the actual implementation should achieve near-optimal candidate recall.

Questions for authors

Given that uniform-weight soft coverage achieves 94.45% pass-any compared with 95.65% for RATTS, how do the authors justify the additional complexity introduced by training and calibrating the reliability model? Could the authors provide a more detailed accuracy–compute comparison against uniform-weight coverage, particularly for final-answer accuracy and total end-to-end inference cost?

3 comments
AuthorsOpenReview ↗

Response to the Reviewer JvLP

We thank the reviewer for their review. Below, we address all their comments.

Regarding the Novelty.

We agree with the reviewer on the methodological contribution. However, as clarified in Appendix A, our contribution is to formulate concept allocation before solution generation and analyze its connection to candidate recall. The proposed method allocates a limited expansion budget among useful, complementary concepts before their solution outcomes are available. The theory supports this formulation by establishing submodularity of candidate recall (Proposition 3.1) and identifying conditions under which the coverage guarantee extends to recall (Theorem 3.3).

Also, while the proposed framework is close to relevance–diversity subset-selection methods, we observe that RATTS achieves a macro-average pass-any accuracy of 95.65%, compared with 94.55% for MMR. The benefit is also visible in the final accuracy, where RATTS achieves 74.42%, and MMR achieves 72.49%. The increase is 1.93 percentage points, which is a substantial improvement. All these comparisons are reported in Appendix D.6 of the revised paper.

Discussion on Theoretical Analysis.

We respectfully disagree with the reviewer on the limited practical value of the theoretical analysis. For instance, Proposition 3.2 gives a computable upper bound on how much another subset could improve coverage at the same budget. When this bound is small, we know that even an optimal selection would not offer a meaningful gain.

Similarly, Theorem 3.3 gives a lower bound on RATTS's retained candidate recall relative to the best subset at the same budget, under the stated success-mode assumption. This bound accounts separately for errors in the weights and similarities. When these errors are zero, the greedy approximation guarantee extends directly to retained recall. And when they are nonzero, the theorem quantifies how much the guarantee weakens. It also shows that the contribution of similarity error to the bound increases with the number of selected concepts.

So while the analysis builds on established submodular optimization results, it helps us understand what we can guarantee from this framework. It gives an upper bound on how much the "best selection method" could improve coverage at the same budget and, under the stated success-mode assumption, a lower bound on how much candidate recall RATTS retains compared with the optimal concept selection at that budget. The bound also tells us how errors in the weights and similarities weaken this guarantee.

Additionally, we add an empirical check in Appendix D.6, under "Coverage and retained candidate recall". Using the stored rollouts, we compare subsets of the same size within each problem and observe that the upper-coverage subsets achieve a retention rate 0.233 percentage points higher than lower-coverage subsets. This provides empirical evidence of a positive relationship between coverage and candidate retention in the evaluated pools. Note that we do not estimate the approximation errors in Theorem 3.3, as it is infeasible to do so in the rebuttal period. However, the theorem establishes how these errors affect the recall guarantee under the stated assumptions, and we will add empirical evidence in the camera-ready version.

AuthorsOpenReview ↗

Response to the Reviewer JvLP [Conitnued]

More details on the accuracy–compute comparison

Compared with uniform-weight coverage, RATTS achieves an observed gain of 2.69 percentage points in final accuracy and 1.20 percentage points in pass-any. These gains come with a negligible additional median time of 48.33 ms and essentially unchanged generation-token usage.

The table below reports a detailed comparison.

QuantityRATTSUniform coverage
Pass-any (%)95.6594.45
Final-answer accuracy (%)74.4271.73
Exploration and expansion tokens per question142,709.8142,828.9
Median complete-selector time in ms per question256.778208.448
Mean end-to-end time in seconds per question312.271312.007

We also see that in the end-to-end time measurement, which includes exploration, selection, solution expansion, and answer aggregation, the observed increase in mean latency is just 0.26 seconds per question, which is approximately 0.08% of the uniform-coverage latency. Thus, the observed improvement in final-answer accuracy comes without increasing the expansion budget and with very little additional end-to-end time in this measurement.

Further, the offline training process is performed only once. Generating the training concept texts produced approximately 190K output tokens for Qwen3.5-9B, 3.07M for Gemma4-E4B, and 565K for GLM-4.7-Flash. For illustration, the same combined number of output tokens would cost less than 20 dollars at GPT-6.1 Sol's current Batch output-token rate. The recorded training runs, including calibration, took between 8 minutes 18 seconds and 15 minutes 55 seconds per scorer. This preparation cost is shared across subsequent inference requests. More details are provided in Appendix D.6 under "Accuracy and computational cost of learned weighting" (Table 16) and "One-time scorer preparation."

We also observe similar macro-average final-answer accuracy when reusing a single scorer across all three generators without retraining or recalibration. Depending on the scorer, accuracy ranges from 74.33% to 74.60%, compared with 74.42% when using a separate scorer for each generator. These results also support sharing the preparation effort across the evaluated generators. This comparison is reported in Appendix D.6 under "Cross-generator scorer transfer" (Table 18).

AuthorsOpenReview ↗

Follow-up on the Rebuttal

Dear Reviewer JvLP,

Thank you again for your review. We believe that our response addresses the concerns raised in your review. As the discussion period is approaching its end, we would appreciate it if you could take a look and let us know if any concerns remain or if any further clarification would be helpful.

Best regards,

The Authors

Comments on the paper

1 comment
AuthorsOpenReview ↗

General Response

We thank all three reviewers for their careful reading and constructive feedback. The comments and suggestions helped us clarify the contribution and strengthen the evaluation. We have uploaded a revised manuscript with the following additions:

  • Positioning and theoretical discussion: Expanded Appendix A to distinguish RATTS from prior allocation methods, including REBASE [1] and DORA [2], and explain the requirements for a controlled comparison.

  • Additional baseline comparisons: Added final-answer accuracy comparisons with uniform coverage, MMR, and Random Cluster, together with comparisons using pretrained PRM scores within the same coverage selector.

  • Computational cost and scorer reuse: Added recorded concept-generation token counts and scorer training times, an accuracy–cost comparison against uniform coverage, and cross-generator scorer-transfer results without retraining or recalibration.

  • Coverage and candidate retention: Added an analysis using stored rollouts to examine whether higher coverage corresponds to a greater chance of retaining a correct solution.

  • Comparisons across budgets: Added pass-any and final-answer accuracy comparisons with MMR and Random Cluster for expansion fractions from ρ = 0.10 to ρ = 0.50.

The additions and revisions are marked in red in the uploaded paper, and our individual responses discuss each concern and question raised by the reviewers. Please let us know if any further clarification is needed from our end, and we are happy to engage in further discussion.

[1] Inference Scaling Laws: An Empirical Analysis of Compute-Optimal Inference for LLM Problem-Solving. ICLR 2025.

[2] Every Rollout Counts: Optimal Resource Allocation for Efficient Test-Time Scaling. NeurIPS 2025.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

Related papers

Loading the map…

Discussion (0)

Sign in to comment.