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- Informativeness
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- Presentation
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- Soundness
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Paper summary
The paper learns long-horizon evolution for PDEs with known scaling covariance by expressing the full solution in self-similar coordinates. Multiplying physical time by a fixed ratio then corresponds to applying an autonomous field-to-field map. MTRG-Fixed learns one residual transition, while MTRG-Variable conditions on the ratio and adds composition consistency; both apply conserved-mass correction during evaluation. The paper establishes the exact composition law and a conditional rollout-error recurrence separating approximation, reference mismatch, and propagation.
Training uses times 1–10, followed by evaluation at 10^2–10^8 using four to sixteen applications. Six analytic-reference benchmarks cover Burgers, porous-medium, fast-diffusion, and heat equations. Seven-seed comparisons and component studies show useful performance on several 1D/2D tasks and benefits from mass correction. Results are weaker on fast diffusion and the small 3D pilot. Analytic limiting profiles outperform all learned methods at 10^8 on the five diffusion benchmarks where they are evaluated; learned full-state evolution helps at some earlier horizons, especially for 2D porous medium.
Critical strengths
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A principled and reusable evolution target. The normalized full-state map follows exactly from scaling covariance, without requiring the input already to be self-similar. This gives a coherent way to learn finite-ratio transitions and reuse them at increasingly distant physical times. The distinction between exact operator structure and conditional learned accuracy is technically sound and consequential to the method's credibility.
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Informative and candid evaluation. Seven-seed results, complete horizon tables, mass/consistency ablations, and analytic-profile controls show both benefits and limitations. In particular, the authors explicitly report regimes where the attractor or another learned mechanism wins. This makes the positive 1D/2D findings more interpretable and avoids equating a large physical horizon with a uniformly difficult prediction problem.
Critical weaknesses
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The central transient-prediction advantage is insufficiently distinguished from low-dimensional profile tracking. Appendix C uses shifted Barenblatt profiles and Gaussian mixtures, with incompletely specified shifts and parameter distributions. Within a shifted Barenblatt family, the future is determined by mass, center, and effective age, whose normalized updates are known analytically. Table 11's 2D heat and porous-medium control errors decay approximately as T^(-1/2) and T^(-1/4), consistent with translation modes. This is a diagnostic observation, not proof of an implementation error. Matched-mass, centroid-aware, and age/width-fitted profile controls are needed, particularly for the sustained 2D porous-medium advantage. Without them or non-Barenblatt nonlinear tests, the evidence for a consequential full-state learning contribution is limited.
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The added computational value over established rescaling methods is not demonstrated. Classical dynamic rescaling already supplies the normalized clock; numerical RG likewise advances and rescales full fields. A relevant missing comparator is Braga et al. (2020), Numerical Renormalization Group Algorithms for Self-Similar Asymptotics of Partial Differential Equations. The physical-time timing comparison combines different rollout lengths with 32,768 versus 256 spatial points, as the authors disclose. The normalized learned comparisons evaluate adapted mechanisms using a common U-Net, rather than the complete source methods. A conventional solver in the same normalized coordinates is needed to establish practical accuracy/cost benefits from learning. This matters because the mathematical novelty is modest and the strongest contribution must come from empirical utility.
Questions for authors
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What are the exact initial-data and analytic-control formulas, including whether the Barenblatt shifts are temporal, spatial, or both, and how the 2D porous-medium center is handled? With identical exact-mass information, how much of the reported advantage remains against centroid-aware and fitted effective-age/width profile controls? Please also explain the absence of a Burgers diffusion-wave control.
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Do the gains persist for nonlinear diffusion initialized away from the Barenblatt family, preferably with mass and centroid controlled? A targeted perturbation test would help establish that the method predicts transient shape changes beyond a few similarity parameters.
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How does MTRG compare in error versus wall-clock cost with a conventional solver in self-similar coordinates or numerical RG on comparable spatial domains and resolutions? What training/setup cost must be amortized? This comparison would separate the benefit of learning from the coordinate and clock transformation.
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Can the authors provide the promised reporting archive and the data-generation, reference, and training configurations needed to reproduce the experiments? In particular, how large are quadrature/truncation and exact-mass-versus-grid-reference discrepancies, and do the principal control comparisons persist under spatial refinement? These details matter for interpreting the small reported errors and the special-family controls.
3 comments
W2 / Q3 — value over rescaling methods and solvers.
W2 / Q3 — value over rescaling methods and solvers. The coordinates, logarithmic clock and renormalization step are classical; the revised draft credits dynamic rescaling and numerical RG (Braga et al., 2020). We did not implement that algorithm and claim no advantage over it, nor over the complete source methods behind our adapted learned comparators. Against a conventional solver in the same coordinates from the same observations (Table S3), we find a task-dependent online accuracy–latency trade-off, not a general saving:
- 2D porous medium: to T = 10² at batch 64, MTRG takes 0.054 s; a 128² finite-volume solve takes 2.6 s and is 3.4× more accurate; a 64² solve takes 0.74 s and is 2.1× less accurate.
- 1D Burgers, same 256 points: a second-order solver reaches 0.13–0.28 % against 1.1–1.4 % for MTRG from T = 10²; we claim no speed advantage.
- Linear heat (separate study, one trained model, 16-step rollout to 10⁸): a conservative solver with mass projection takes 7–8 ms per batch against 54–91 ms for MTRG, with a largest horizon-mean error of 0.09 % against 0.52 %. The solver is cheaper and more accurate.
Timings are recorded for research implementations on one GPU type (FP32 network, FP64 solver), with no optimized solver. Offline cost counted: 4.3 GPU-hours of training references and 90 s of training for one model; validation and test references, pilot runs and development time are not counted. As conditional arithmetic on implementations of unequal accuracy, this equals the measured online difference after ≈ 3.9·10⁵ porous-medium trajectories to T = 10² at batch 64. The revised draft states that the timings do not establish a general computational advantage. It adds one motivation, stated as untested: inference never evaluates the differential operator, so training could in principle use observed trajectories when the scaling law, state, time labels and invariant are available.
Q1 — Burgers diffusion-wave control & Q4 — numerical reliability and reporting materials.
Q1 — Burgers diffusion-wave control. The submitted comparison omitted it; we added limiting, least-squares-fitted and moment-matched diffusion waves (Table S7). At T = 10² MTRG has the lower cohort mean (1.2 % against 20.8 %, 9.35 % and 16.4 %), but the moment-matched wave is more accurate on 86 % of trajectories, and all three waves overtake MTRG from T = 10⁶. The Cole–Hopf formula agrees with the reference to rounding on these data, so this benchmark shows no advantage over an analytic solution.
Q4 — numerical reliability and reporting materials. For the new porous-medium references (Table S11): N = 512 differs from N = 1024 by ≤ 2.4·10⁻⁴ for T ≤ 10², and from the exact elliptical solution by 1–2·10⁻⁴ on average through T = 10⁸; halving the time step changed one pilot family by ≈ 10⁻¹⁰ (T ≤ 10²). These are measured discrepancies, not error bounds. Our decision threshold is three times the larger grid-refinement discrepancy (raw discrepancy ≤ 8.8·10⁻⁴, so 0.14–0.26 percentage points); this applies to the porous-medium comparisons reported above as resolved; lower means and crossover locations are descriptive. The mass label equals the cell-area-weighted sum of the observation to rounding, and no mass reaches the outer ring of the computational box; we did not vary the box size, and these checks do not extend to the submitted benchmarks. We have prepared a reporting archive for the new studies: saved per-seed and per-trajectory errors, recorded timings, configurations, recorded summaries, and scripts that regenerate the supplementary tables and the figure from these metrics and explicitly identified recorded summaries. It does not retrain models, regenerate trajectories, remeasure timings or re-execute field-level checks. We are not able to provide the seed-level archive for the submitted tables that the original reproducibility statement describes; the revised statement describes only what is available.
W1 / Q2 — full-state prediction versus profile tracking & submitted controls, centre and age; formulas.
We thank the reviewer for a precise diagnosis. We ran the two tests it asks for: nonlinear diffusion away from the Barenblatt family with matched information, and a conventional solver in the same coordinates. They are supplementary experiments (separately implemented pipeline; five training seeds unless noted); they neither replace nor reproduce the submitted tables. They support a narrower empirical claim than the submission's, and the revised draft states it.
W1 / Q2 — full-state prediction versus profile tracking. New experiment (supplementary; Appendix D.2): 2D porous medium with initial data that are sums of 2–4 anisotropic compact bumps; 1,024 training trajectories supervised only at t = 1 → √10 → 10; 64 independent test trajectories; five training seeds. Every method receives the same 128² initial cell averages, whose cell-area-weighted sum is the exact mass. We compare with six initial-only fitted-profile controls (Table S12). The strongest at every horizon is the elliptical quadratic-pressure solution family fitted to mass, centroid and covariance: a known-form solution of the equation, though not the exact evolution of a multi-bump field. Mean relative L² error:
At the two supervised horizons and at T = 10√10, the first tested time beyond the window, MTRG is 7×, 4.5× and 2.2× more accurate than the strongest control, in all five seeds. At T = 10² the difference is unresolved. From T ≈ 3·10² the profile is more accurate and remains so, and the same-grid solver is 3–7× more accurate than MTRG at every tested horizon (all 16 horizons: Fig. S1, Table S5). The supported claim is finite-time predictive value beyond the six tested controls, not a statement about every low-dimensional representation and not sustained late-time superiority. Out of distribution (Table S6), the advantage holds for 5–6-bump data through T = 10²; for flat-topped data as a whole it is established only at √10.
W1 / Q1 — submitted controls, centre and age; formulas. We agree that the submitted comparison (Table 11) does not isolate full-state utility against centre-, age- or covariance-aware controls. In the new experiment the mean-error crossover location depends on the control: about 3·10⁷ for a centred limiting profile that does not track the centroid, 3·10³–10⁴ for a centroid- and age-matched isotropic profile, and 10²–3·10² for the elliptical family. These are where the mean errors cross; the change of ranking is resolved under our rule only from 10⁸, 10⁴ and 3·10² respectively. Untracked translation can thus produce a prolonged apparent gain of the kind the reviewer inferred. We do not claim that this explains the submitted Table 11 numbers, and we cannot add detail on the Barenblatt shifts or the 2D centre handling of the submitted runs beyond what the manuscript states. Within a correctly specified analytic family a fitted profile describes its own trajectories without full-state learning, so Barenblatt-family benchmarks cannot separate the two. The revised draft says so, removes the sentence about a sustained interval of advantage, and adds the horizon-limited comparison with fitted controls (Section 5.2, Table S5). Initial-data formulas, parameter distributions, centre and age definitions and fitting objectives of the new study are in Appendix D.2 and Table S12.