- Table 1 reports Naive Async success of 82.60% at d=0, followed by 82.35%, 82.20%, and 82.85% at d=1,2,3. Thus, baseline success is essentially flat rather than showing a systematic decline as delay increases. TRACE averages 82.85% versus 82.47% for Naive Async over the positive delays, a difference of only 0.38 percentage points (23 additional successful evaluations over 6,000 task–state–delay instances). Such a small aggregate difference does not by itself establish a reliable improvement. Paired uncertainty estimates and per-task analyses are needed, particularly because the same tasks and initial states are reused across delays. Appendix D also records a two-success difference between the two nominally equivalent zero-delay runs (1,652 versus 1,650 out of 2,000), reinforcing the need to quantify run-level variability rather than to interpret small differences without uncertainty quantification.
There is a specific reporting concern: Appendix D states that the completed 20,000-episode LIBERO evaluation covered d=0,…,4, yet the main result tables report only d=0,…,3. The d=4 full-cohort results should be provided, with an explanation for their omission. Appendix C's five-state d=4 sensitivity results are not a substitute for the matched 50-state comparison. The model is trained with delays as large as d=10, but the principal evaluation covers a much narrower range. Under the paper's single-worker schedule, d≤R=5; d=5 could therefore be tested at the existing stride, whereas larger delays would require a changed stride and appropriately matched baselines. Finally, LIBERO compares only against Naive Async, not an RTC-style or other appropriate delay-aware VLA baseline. This makes the method's advantage over existing asynchronous compensation strategies unclear.
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A central motivation is that Pt specifies intended future commands but not their realized effects, so history Hts and Htv should provide complementary information. Yet no reported closed-loop comparison independently removes history, removes the committed prefix, or tests their combination. Appendix C.1 states that the Kinetix controls do not remove history or isolate the encoder architecture, and Appendix C.2 confirms that the LIBERO history-content controls were paused before training. As a result, the Kinetix gain over Hard masking could arise from learned prefix conditioning, historical observations, the combined adapter capacity, or their interaction. The separate contributions of the Kinetix residual regularizer Lres and LIBERO displacement loss Ldisp are likewise untested in matched closed-loop ablations. The offline visual-feature comparison in Table 14 is informative but does not demonstrate improved closed-loop success.
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The paper correctly states that the reported delays are simulated action-availability offsets, independent of measured inference time. This separation is useful experimentally, but it leaves the real-time deployment claim incomplete. On LIBERO, TRACE adds approximately 16.88M trainable parameters, including multiple temporal encoders and six residual-injection layers used during ten Euler steps. On Kinetix, guided sampling also uses a VJP through the adapted endpoint predictor. The paper does not provide wall-clock chunk-generation times, additional encoding and injection costs, GPU utilization, or deadline-miss rates relative to the corresponding baselines. If the added computation changes the achievable inference-to-takeover delay, comparing both methods at the same simulated d may overstate the realized advantage. A latency-aware comparison should report success at the respective measured delays under the same hardware, batching, and queueing conditions.
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Both adapter instantiations are trained using a single reported training seed. Kinetix uses a distinct evaluation episode-seed cohort after calibration, which supports confirmation of the selected configuration but does not measure retraining variability. On LIBERO, the reference recipe was selected using initial states 0–4, which are then included in the 0–49 main evaluation; this does not invalidate the results, but it means the full cohort is not strictly untouched by model selection. Moreover, the released frozen backbones had already been trained on the source demonstration corpora, so the adapter-held-out episodes are not necessarily unseen by the complete system. These facts warrant a more precise statement about the scope of generalization and, ideally, validation across adapter training seeds and an untouched evaluation set. They do not by themselves establish data leakage or explain the increase in late-training MSE.