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- Informativeness
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Paper summary
The paper argues that an incoherent tensor power-summed operator F₂ is more faithful than a coherent scalar operator F₁ for NV relaxometry inversion. It diagnoses a “center collapse” of free-density solvers under F₂ and proposes NeTMY, a per-instance coordinate neural field whose parameterization filters the density gradient through a PSD kernel G_θ = J_θJ_θᵀ (Lemma 2). Evidence comes from an F₃-generated 512-sample cross-fidelity benchmark, matched-operator benchmarks, and an 8-NV α-RuCl₃ cross-check.
Critical strengths
The forward-model gap is spelled out explicitly (Eq. 12), and the failure mechanism has measurable diagnostics (iter-0 center/outer ratio 18.29× vs 1.6×; SVD energy split). The paper also reports unfavorable results (the F₂→F₁ cross, PnP/RED, failure modes). This makes the experimental setup more credible. The mathematical derivations are correct, though fairly basic.
Critical weaknesses
Weaknesses
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- The collapse mechanism is not separated from the choice of loss and optimizer. ω_L is a per-pixel unknown field (B.7), constant only within each ground-truth source (line 1471), and the Lorentzian γ²/((ω − ω_L)² + γ²) is nonlinear in ω_L (Eqs. 2–3), so the joint (ρ, ω_L) problem is generally non-convex. For a fixed ω_L, however, the unnormalized F₂ is linear in ρ (line 1314). The diagnosed collapse (peak coupling plus first-step center bias) is tied to two design choices: log-MSE on max-normalized maps, and Adam from a uniform start. Please add a diagnostic: with oracle ω_L (or alternating ω_L updates), solve for ρ with NNLS or non-negative ℓ₁ (FISTA) and compare on the primary metrics. Please also report free-density controls with random initialization and with an unnormalized linear loss. This is only a diagnostic, since oracle ω_L + NNLS changes the information available, the loss and the solver at once. If it also collapses, the mechanism claim is strengthened; if not, these three factors need to be controlled separately (e.g., oracle ω_L with the normalized log-MSE and Adam) to locate the cause. Separating the mechanism correctly would make the conclusions deeper.
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The three real-data axes disagree, and the main text should present them evenly. The main text reports the depth-amplitude and conditioning axes, points to the slope axis in F.10, and qualifies the conclusion to those two axes. On the slope axis the measured value is b_exp = 1.43 ± 0.21. Treating the reported ± as standard deviations, assuming independent errors and propagating α = 1.06 ± 0.22 to first order gives 1.89 ± 0.39 for F₁ (~1σ away) and 3.77 ± 0.78 for F₂ (~2.9σ away). This is an order-of-magnitude estimate, not a formal test. Meanwhile, F₂ also fails 7/8 NVs on depth-amplitude, and Hessian conditioning under a Gaussian ansatz measures identifiability rather than correctness. The 8-NV data therefore do not discriminate between the operators, and the axis that directly tests the scaling is closer to F₁. Please report all three axes side by side in the main text, including the prediction uncertainty.
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The tables are inconsistent and the statistics are unclear. Table 9 is a 128-scene subset of Table 1's benchmark. Its F₁ columns match Table 1, but its F₂ MSE column differs by two to three orders of magnitude: NeTMY 4.46 vs 0.0078, Tikhonov 1.13 vs 0.0082. The authors note that Table 9 consists of reruns on the subset (line 1578) and that means exceed medians, which does not account for a gap of this size. Possible sources include the subset composition, the rerun settings and the MSE scale correction (Eq. 30); please explain.
Some intervals in Table 1 (“95% CI across 3 seeds”) are very wide with negative lower bounds (Tikhonov F1 0.465 ± 0.436; ADMM MSE 3.84 ± 4.97), although Tikhonov is deterministic. Please state whether the intervals are computed across seeds or across samples, and add the paired bootstrap comparisons already used in F.6. The ablation (Table 3) uses MSE/SSIM rather than the primary metrics, and its protocol is not stated. The full-model MSE of .0039 is close to the F₂/F₂ value in Table 2, which suggests a matched-operator setting. Please state the protocol and report the ablation on the F₃→F₂ benchmark with the primary metrics.
- Baseline tuning is unequal. NeTMY's hyperparameters are swept on held-out data (Table 13). Tikhonov's and ADMM's regularization weights are fixed, with Tikhonov's explicitly set to NeTMY's values, and ADMM uses a different Larmor construction. This makes the comparison clearly unfair; I hope the authors align the settings for a fair comparison, which would substantially strengthen the paper's credibility.
Minor comments
- The supervised baselines are trained on dense scenes and tested on sparse ones, although sparse training pairs are free to simulate; a distribution-matched amortized baseline is needed, especially given the 2.6-query compute crossover.
- The runtimes in Table 8 (780 s, A6000) and Table 14 (141 s, L40) use different protocols.
- ADMM and DeepDecoder give near-identical F₂/F₂ MSE (0.2555/0.2558); please explain.
- Cite the concrete prior equations or code that use F₁.
- The scope (2-D, single 20 nm standoff, 64×64 grid) should be stated in the abstract.
Questions for authors
(1) With oracle (or alternating) ω_L, do NNLS or non-negative ℓ₁ also collapse? (2) What are the slope-axis deviations once the uncertainty of α is propagated, and can all three axes be reported in the main text? (3) What explains the ~570× gap between the F₂ MSE in Table 9 and Table 1? Are Table 1's intervals across seeds or across samples, and which operator setting does the ablation use? (4) Does the ranking change when the baselines receive equal tuning?