- Rating
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- Confidence
- 4
- Informativeness
- 2
- Presentation
- 3
- Soundness
- 1
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Paper summary
PairTrans addresses a SCD problem and shows improvements in the low-data settings on three datasets among five architectures. A SCD augmentation pipeline is clearly formulated as bidirectional source-conditioned target-side generation from real annotated pairs that enhances the method understanding.
Critical strengths
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PairTrans show practical significance for SCD problem. Since obtaining paired annotations for semantic change detection is costly, it is worth investigating how to generate training data from a limited amount of real-world paired data.
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The experiments encompass multiple downstream architectures, suggesting that the utility of the proposed method.
Critical weaknesses
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The novelty should be clearly discussed. The distinctive contribution appears to be the conditioning arrangement built around a real annotated pair. The two-stage semantic-to-visual pipeline and the underlying diffusion-conditioning mechanisms largely build on existing approaches (https://arxiv.org/abs/2503.15683).
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The formulation does not adequately explain how it handles the datasets’ annotation conventions. Sec. 3 assumes complete land-cover maps and defines changed area through semantic-label inequality in Eq. (6) and (16). However, SECOND explicitly distinguishes unchanged pixels from changes within the same land-cover category, such as building demolition and reconstruction. Its annotation convention therefore cannot be fully represented by label inequality alone.
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The connection between transition-matrix perturbation and the final synthetic supervision is insufficiently validated.
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The comparison with real-only training confounds augmentation with additional optimization. All downstream models are trained for 50 epochs, while augmentation increases the dataset size by a factor of six under the 1:5 real-to-synthetic ratio.
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PairTrans improves binary F1 and F_{scd} but reduces Score and SeK relative to real-only training across all five architectures. The authors appropriately acknowledge this trade-off, but do not analyze its cause.
Questions for authors
Since PairTrans only employs remote sensing datasets in the main experiment, how well does it generalize to street-view or SAR data?
2 comments
Thank you again for your careful review. As the discussion period ends soon, we wanted to check whether our response and the revised manuscript address your concerns. If so, we would be grateful if you would consider updating your score. We are happy to clarify anything else before the deadline.
Response to Reviewer Ejnh
We thank the reviewer for the thorough review. In short:
All changes are marked in red in the revised PDF.
W4. Training-budget confound.
We agree that the fixed-epoch protocol gives augmented runs more updates. We therefore trained real-only for the same 5,550 updates that PairTrans receives in 50 epochs on the 1:5 set, about 300 epochs over the real pairs (Appendix C.1, Table 15):
The additional updates do not improve real-only training on average, and PairTrans stays higher on every backbone, by 1.09–3.01 Score. HySCDG, with the same synthetic volume and budget, falls below real-only training on all five backbones (Table 16), so more samples or steps alone do not explain the gain. This control covers SECOND; the Evaluation Scope paragraph now notes that Landsat-SCD and HiUCD still use the fixed-epoch protocol.
W3. Transition-matrix validation.
We added this validation (Appendix C.4; see also our reply to HVXA).
As one seed sets both the request and the noise, this shows association, not a controlled intervention.
W1. Novelty and relation to HySCDG.
We agree that two-stage semantic-to-visual generation and diffusion conditioning are not our contribution. The contribution is reciprocal source conditioning: each endpoint of a real pair conditions the opposite side, with target semantics proposed from the pair's directed transition matrix. The two directions form a pair with two generated endpoints.
HySCDG instead edits only man-made object instances of a densely labeled single-temporal map, following its released code (Appendix A.3.3), and forms one-real-one-generated pairs. In our experiments:
HySCDG is added to Table 1 and the related work.
W2. Annotation conventions.
We agree that label inequality cannot represent SECOND's same-class changes, such as building reconstruction. Our setting follows the baseline ChangeDiff, whose released code defines change as
pre_target != post_targetin training and evaluation; we use this code unchanged for all methods and datasets, consistent with Eqs. (6) and (16). Same-class changes therefore count as unchanged for every method, so all comparisons share one convention. Sec. 4.1 and Appendix A.5 now state this, and Appendix A.1.1 describes the SECOND annotations accordingly.W5. Score and SeK on HiUCD.
We agree that this trade-off needed an analysis; Appendix C.7 (Table 23) now provides it. Only 1.56% of the HiUCD test pixels change. SeK removes true negatives but keeps the chance term FP·FN/(N−q₀₀)² of the unchanged class. With fewer false alarms, this term rises (A2Net: 0.056 → 0.113), and SeK decreases although the predictions improve. A model that predicts (almost) no change gets SeK ≈ 0, as real-only SSCDL and BiSRNet do. Kappa, which keeps true negatives, is highest for PairTrans on all five backbones:
Among all compared methods, PairTrans also has the highest mIoU, Fscd, IoU, and F1 on all five backbones (Table 14). Sec. 4.2 now states this.
Q1. Street-view or SAR data.
The transition and mask stages operate in label space and do not depend on the sensor; the pipeline already spans 0.1 m to 30 m optical imagery. Street-view and SAR also require adapting the image generator and class space and training on new data, which was not feasible within the rebuttal period. We therefore focused the new experiments on our existing benchmarks and will complete the street-view and SAR training and evaluation after the rebuttal.
We hope the added analyses address the reviewer's concerns.