acceptodds
Under review as a conference paper at ICLR 2027

When the Display Is Wrong: Concept-Dependent Compensation in World-Model Agents

Abstract

A world-model agent may retain task information when its observations become misleading, but whether that information sustains control requires a causal test. In Craftax-Classic, we falsify inventory counts without changing actual resources. We compare four -IRIS agents, whose policies receive frames, with ten DreamerV3 agents, whose policies receive recurrent and stochastic world-model states; all were trained with visible inventory. A false zero stone count reduces stone-related achievement rates from to in -IRIS, but only from to in DreamerV3. This preserved performance motivates a within-agent test of recurrent support. Removing a readout-defined recurrent stone subspace has little effect with an accurate display but substantially increases impairment when the display is false. Replacing that component with one from a recorded donor state largely restores performance when the donor's resource status matches the agent's actual inventory; wrong-status donors do not. The correct-donor advantage grows from percentage points with an accurate display to with a false display, an increase of points (Holm-corrected ). Wood interventions are individually costly, and newly trained probes still decode resource availability after projection, limiting generalisation across resources and ruling out complete information erasure. However, correct- and wrong-status patches differ both in the magnitude of the recurrent-state change they induce and in their contextual similarity to the receiver, so restoration cannot be attributed solely to resource information. The results support partial recurrent compensation for misleading sensory input in the tested DreamerV3 agents, while the wood comparison shows that this capacity cannot be assumed for every resource represented by the same world model.

Primary area:
interpretability and explainable AI
Keywords:
mechanistic interpretability, world models, model-based reinforcement learning, causal interventions, recurrent representations

Reviews

Among:
Shape:
1234this paper, Bottom 9%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.40 over 5 reviews, above 9% of the others.
Reviewer_tDqtOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
1
Soundness
2
Read review
Paper summary

This paper studies whether recurrent representations help world-model agents compensate for misleading observations in Craftax-Classic. The authors falsify inventory displays without changing actual resources and compare Δ-IRIS and DreamerV3, followed by within-DreamerV3 recurrent-subspace ablation and donor-state replacement. Removing the selected stone-related component causes greater impairment under a false display, while correct-status donors restore performance more effectively than wrong-status donors. Validation includes simulator-recorded achievements, paired agent-level comparisons, multiplicity correction, and additional probing and repair experiments. The findings support conditional recurrent involvement in behavior, while residual decodability and differences in donor-patch magnitude and context limit resource-specific mechanistic attribution.

Critical strengths
  • Informative crossed-intervention design: Combining display falsification with recurrent-state ablation uncovers conditional behavioral effects that isolated interventions miss, showing consistent negative interactions across all ten DreamerV3 agents.
  • Direct behavioral validation: Grounding evaluations in simulator-recorded achievements rather than model predictions—paired with matched initial states and multiplicity correction—ensures high empirical credibility.
Critical weaknesses
  • Unresolved mechanistic attribution: Correct- and wrong-status donor patches differ in perturbation magnitude, context similarity, and collateral impact on non-target features (e.g., wall coordinates), with norm matching failing predefined criteria. Performance recovery cannot be cleanly attributed to resource content.
  • Limited explanatory scope: Strong compensation effects appear only for stone tasks across ten DreamerV3 agents in a single environment. Results for wood, stochastic repair, and policy relearning remain inconclusive, offering only a narrow view of recurrent compensation.
Questions for authors

Q1: Does the performance advantage of the correct donor persist when perturbation magnitude, wall status, and other non-target attributes are jointly matched between patches?

Q2: Does the stone-related interaction hold when stone-tool crafting and stone placement are evaluated separately, especially given the donor patches' collateral impact on wall representations?

Reviewer_gC4QOpenReview ↗
Rating
1
Confidence
4
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

The paper falsifies a single inventory count on the Craftax-Classic HUD and investigates whether a world-model agent's latent state can sustain behavior when its observations become unreliable. The comparison is motivated by a striking difference in robustness: falsifying the stone count nearly eliminates stone-tier achievement for Δ-IRIS (4 agents) but has little effect on DreamerV3 (10 agents).

Critical strengths

The core design matches the hypothesis. The authors recognise that a component made redundant by another source can appear unimportant under isolated lesions, and they design the experiment to expose this. Crossing a recurrent-state projection with a falsified observation is a clean way to reveal conditional importance. The resulting interaction (I = −0.268, negative in all ten agents) is large and consistent. The design should be reusable for finding hidden dependencies in other agents.

Claims are calibrated to the evidence. The paper consistently limits itself to “partial compensation.” It explicitly declines Boolean-circuit, erasure and autonomous-reconstruction readings, and it raises the patch-magnitude and wall-status confounds itself. The wood result, which does not show the stone pattern, is reported and used to bound the claim rather than omitted.

Critical weaknesses

Weaknesses

My primary (and strong) concerns relate to the design and interpretation of the interventions on the V3 RSSM architecture. I largely agree with the author's premise, and believe the topic to be quite relevant.

1. State intervention and information removal.

The state intervention seems to be dependent on the logistic probes that were trained, it is not clear whether P_W h actually does remove information with h with respect to the decoder, policy, or learned bias. Fresh probes are done repeatedly, but the False display appears to be the true removal for only the current time step, and even then newly trained probes can still recover the stone. For a false display and h kept/projected, does the current h_t encode a history of false displays? I am not convinced that this is a proper way to remove information from h_t and not expect other components to be disrupted.

2. Limitations of the Δ-IRIS comparison.

The Δ-IRIS comparison uses only four agents and does not appear to include a corresponding intervention test, limiting the strength of the evidence. Moreover, no recurrent-state intervention is performed on Δ-IRIS, so the comparison cannot directly test the proposed mechanism.

More substantively, the paper states that Δ-IRIS "acts directly on observed frames." However, my understanding is that IRIS-family actor-critic architectures use a CNN followed by an LSTM to process observations over time, meaning the policy itself has recurrent memory. If this understanding is correct, the contrast is not between a memoryless frame-based policy and a recurrent latent-state policy. The authors should clarify this architectural distinction and explain what specifically differentiates the agents' memory mechanisms in this experiment.

3. Justification and interpretation of donor patches.

The motivation for the donor-patch intervention is unclear. As I understand it, a donor patch projects a donor latent state onto the subspace PWhP_W h identified by the probe and adds that component to the current latent state. However, it is unclear whether this intervention preserves consistency between the current observation xtx_t and the resulting latent state hth_t.

In particular, is the patched latent state passed through the GRU to produce ht+1h_{t+1}, which is then combined with the next observation embedding zt+1z_{t+1} derived from the unmodified environment? If so, the intervention could introduce a mismatch between the recurrent state and subsequent observations. How do the authors establish that this does not create conflicting information within the world model? More generally, how can they distinguish the intended effect of injecting donor information from potential artifacts caused by inconsistencies between hth_t and ztz_t?

Without addressing these questions, it is difficult to determine whether the donor-patch results provide evidence for the proposed mechanism or reflect the effects of an internally inconsistent latent state.

Questions for authors

See weaknesses

Reviewer_LjaEOpenReview ↗
Rating
1(−1)
Confidence
4(+1)
Informativeness
1
Presentation
1
Soundness
2
Read review
Paper summary

The paper studied whether the world model agents can use their internal representations to correct for misleading observations. To this end, the authors compared Dreamer V3 and Δ\Delta-IRIS in Craftax by falsifying displayed inventory counts without modifying the underlying environment state.

The author studied it using supervised probing, and subspace projection. Their try to use the experimental results to support that the agent behavior can be corrected by their internal state when the external observations are misleading.

Critical strengths

First of all, I thoght the empirical observation is interesting, the paper shows that the relationship between internal world model representations and agent behavior under misleading observations, which is very different from the standard study settings.

The ablation study is extensive, the authors conduct a relatively comprehensive set of experiments.

Critical weaknesses
  1. From my view of point, the motivation of the study is limited, and the practical significance is unclear. Although the observations are interesting, the paper does not successfully establish why investigating this particular compensation phenomenon is important for world-model applications. The evaluation is limited to failure case in Craftax. It is unclear whether the it generalizes to more realistic settings or provides meaningful benefits for practical decision-making systems.

  2. The comparison with existing methods is insufficient, making it unclear whether the phenomenon investigated in this paper represents a significant and unresolved challenge in the literature. A more systematic comparison with established causal intervention and representation-analysis approaches would help clarify the methodological novelty and practical significance of the proposed method. In particular, it would be valuable to examine whether alternative methods for identifying or removing concept-related representations yield similar findings, and to what extent the proposed approach offers advantages over these alternatives.

  3. The writing is difficult to follow due to its complicated experimental organization and dense presentation of technical details. Multiple experiment identifiers, appear throughout the main text, requiring frequent reference to the appendices to understand the relationships between experiments.

  4. the authors cited [1], however, this work primarily investigates post-hoc concept control in generative models, rather than state representations in reinforcement learning agents.

[1]. Akshay Kulkarni, Ge Yan, Chung-En Sun, Tuomas Oikarinen, and Tsui-Wei Weng. Interpretable generative models through post-hoc concept bottlenecks. In IEEE/CVF Conference on Computer Vision and Pattern Recognition, 2025. URL https://openaccess.thecvf.com/ content/CVPR2025/html/Kulkarni_Interpretable_Generative_Models_ through_Post-hoc_Concept_Bottlenecks_CVPR_2025_paper.html.

Questions for authors

Please add a discussion section of real-world applications and practical implications. I recommend revising the manuscript to address these concerns before resubmission.

Reviewer_oGbqOpenReview ↗
Rating
3
Confidence
3
Informativeness
3
Presentation
2
Soundness
2
Read review
Paper summary

The paper studies whether recurrent state in a world model helps an agent act when its current observation gives misleading inventory information. In Craftax-Classic, the authors replace a displayed resource count with zero without changing the simulator's actual inventory. Stone achievements almost disappear in the four evaluated Delta-IRIS agents, while the ten evaluated DreamerV3 agents trained with the HUD visible remain largely successful. The main mechanistic test is within DreamerV3: projecting out a recurrent stone subspace defined by readouts has little effect with an accurate display, but becomes much more disruptive when the count is false. Replacing that component with a donor state carrying the correct status restores much of the lost performance; donors carrying the wrong status do not. Further experiments examine wood, residual decodability, actor versus transition access, repair of the stochastic state, and policy retraining. The authors conclude that the tested agents show partial recurrent compensation, while leaving the specific resource mechanism unresolved because donor patches differ in magnitude and context.

Critical strengths
  1. The crossed intervention answers a question that an isolated ablation would miss. With the normal stone display, recurrent projection changes success only from .980 to .974. Under display falsification, the same operation brings success down to .665, and the interaction is negative in all ten evaluated DreamerV3 agents. This is much better evidence for a conditional behavioral role than either successful decoding or preserved performance under a false display alone. The simulator's resource state stays intact, a sham redraw controls the procedure for editing pixels, and outcomes come from simulator achievements rather than a learned detector. Starting states verified by hashes and matched rollout randomness also make the contrasts within each agent easier to interpret. I put substantially more weight on this experiment than on the comparison between architectures, where the policy interface is not the only difference.

  2. The additional experiments clarify what the intervention does and does not establish. Under the false stone count, patches with the correct status raise success from .665 to .923, whereas patches with the wrong status give .660. The increase in the advantage of correct donors is similar across three seeds used to select donors. At the same time, newly fitted probes still recover stone availability after projection, with AUROC .997. That result rules out the tempting interpretation that the intervention erased the concept. Wood behaves differently, and the failed positive control for stochastic repair is correctly treated as leaving the stochastic mechanism open. Restricting wood repair to the actor or to the transition is also useful: supplied recurrent state can affect both immediate action selection and later state updates. These checks make the paper informative even though they do not explain the behavior through a single feature.

Critical weaknesses
  1. The donor contrast does not isolate resource content, and the remaining alternative is closely tied to the measured outcome. The keys for selecting correct and incorrect donors do not equally constrain whether the agent faces a wall. Success at the stone tier is dominated by placing stone, which itself depends on the faced cell. Appendix K reports that, for receivers holding stone, offline agreement on wall status is 100% for correct donors but 58.2% for wrong donors; the independent readout for the faced cell also changes more under patches with the wrong status. Thus, the patches can differ in information directly relevant to the placement decision, not just in stone availability. Patch magnitude is another confound. The experiment selecting donors by norm was attempted, but failed its predefined matching criterion, and the more similar aggregate norms do not establish matching at each step along diverging trajectories. I appreciate that these limits are stated in the abstract and discussion. Nevertheless, they leave a real distinction unresolved: the observed interaction could reflect recurrent support relevant to the task without demonstrating compensation specifically through information about resource status. Some appendix wording, including statements that recurrent stone content is used when the HUD is wrong, should be brought into line with that distinction.

  2. The historical provenance record has substantial gaps, which makes the reproduction status of the final primary experiments important to clarify. Appendix N reports 555 distinct output files, with generating commits missing for 321; 142 of the files that do record a commit were generated with unrecorded changes in the working tree. This matters because several corrections changed the intervention object or the interpretation, including the deficient rank of the stone basis and validation of a refitted rather than deployed subspace. The instrumented reruns are encouraging, and missing historical commits are not evidence that the current results are wrong. Still, regenerating figures from committed aggregates is different from regenerating the primary contrasts from a fully specified source state. I would like a compact reproduction path for F4/F4R and validation of the deployed intervention, with exact configurations, required checkpoints and corpora, and the corresponding output hashes. Preserving every unsuccessful historical run is less important than making those final experiments reproducible. I assessed the manuscript and appendices, not the accompanying code, so this is a request for clarification rather than a finding that the release cannot reproduce the result.

Questions for authors
  1. Can the existing F4R records separate the contrast in donor status from compatibility with the faced cell? Please report the contrast on any sufficiently supported subset where both donor types match the receiver's wall status, and distinguish measurements along the trajectories from the offline donor diagnostic. If the current records cannot support that analysis, would you agree that the demonstrated result is conditional use of a recurrent subspace relevant to the task, rather than identified compensation through information about stone availability? I am not requesting a new benchmark; the answer would determine how specifically I interpret the rescue.

  2. Which primary results have been rerun from a clean, recorded source revision with the final basis obtained through rank revelation and the exact deployed donor rule? In particular, can F4R's four primary contrasts and the intervention validation be reproduced from the supplied artifacts without relying only on committed aggregate tables? Please identify the minimal reproduction entry points and any unavailable dependencies.

Reviewer_cZpkOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper investigates whether recurrent world-model representations support agent behavior under misleading observations. In Craftax-Classic, the authors falsify displayed inventory counts and intervene on readout-defined recurrent subspaces in DreamerV3. Removing a stone-associated component has little effect with an accurate display but substantially impairs performance when the display is falsified. Correct-status donor patches largely restore performance. The display-conditional compensation pattern holds for stone but not wood, although the interventions do not isolate resource information from other state properties.

Critical strengths

The crossed display-by-recurrent-state design is well motivated and demonstrates how isolated ablations can underestimate conditional importance. The correct-versus-wrong donor comparison strengthens the causal analysis, with consistent results across three donor-selection seeds.

I particularly appreciate the simulator-scored outcomes, paired rollouts, agent-level statistical inference, and distinction between decodability and causal use. The authors also validate deployed interventions through instrumented reruns, examine actor-versus-transition repair pathways, include sham-redraw controls, and use TOST with a predeclared equivalence margin. Their disclosure of unsuccessful controls and corrected analyses is commendable.

Critical weaknesses
  1. Resource availability is entangled with action affordances. The stone subspace includes readouts for availability, craftability, and placeability. Since placeability depends on the faced cell and place_stone dominates the success endpoint, the intervention may alter action-feasibility information rather than resource belief alone. Could the authors repeat the compensation experiment using an availability-only subspace, with a suitable dimensionality or perturbation-magnitude control?

  2. Donor-selection confounds limit the content-specific interpretation. Correct- and wrong-status patches differ in magnitude and contextual compatibility, including faced-cell status. The norm-matching attempt did not meet its predefined criterion. Appendix J further shows that selected wrong-status donors improve success from 0.660 to 0.802 despite retaining the incorrect resource status. Notably, these selected donors induce larger patches, so neither perturbation magnitude nor resource status alone explains the results; donor identity and context appear important. A better-matched donor comparison or sensitivity analysis would strengthen the causal attribution. A random rank-3 subspace donor-patching control would also help establish whether the readout-defined subspace has a privileged role, especially given the high residual decodability after projection.

  3. The stone–wood comparison confounds resource identity with task structure. After the first collection, stone placement is immediately feasible, whereas placing a table generally requires collecting another wood resource. The wood condition therefore imposes additional collection and memory demands. Starting wood evaluations after the second collection would offer a more comparable test. Additionally, a stone-availability readout on unpatched false-display trajectories would help distinguish persistent inventory representations from recent-collection traces.

  4. Scope and architectural interpretation remain limited. The Δ-IRIS versus DreamerV3 comparison involves only four selected Δ-IRIS agents and does not isolate the effect of the policy interface. Does the Δ-IRIS actor–critic in this implementation have its own recurrent memory? If so, the relevant distinction concerns access to world-model state versus recurrent policy memory more generally. The findings also concern selected agents in one environment, limiting broader claims about compensation across world-model agents.

The manuscript would also benefit from a more focused narrative separating the original architecture investigation from the compensation experiments. A clean, tagged reproduction of the primary F4/F4R results would strengthen the otherwise commendable reproducibility record. The broad interest of this work and its novelty seem limited, with the work predominantly focussing on largely behavioural, non-theoretically motivated, interpretability analyses of a specific domain.

Questions for authors

The highest-priority additions are (i) an availability-only intervention, (ii) better-controlled donor comparisons, and (iii) direct measurements of recurrent inventory information under the false display. The matched wood experiment would further strengthen the concept-dependence claim.

Overall, this is a thoughtful causal investigation that convincingly demonstrates conditional recurrent-state importance. The remaining question is whether the specific resource-information mechanism proposed to explain compensation is adequately identified and is applicable to a more general class of models. I would be receptive to targeted additional evidence in the authors' discussion, and discussion that places their results in broader context.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

Related papers

Loading the map…

Discussion (0)

Sign in to comment.