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Paper summary
This paper studies the stopping mechanism with risk control in iterative systems, where predictions may be revised over multiple iterations. Authors consider three policies: taking action based on the current prediction, continuing reasoning, or postponing the decision. The goal is to maximize the degree of automation while limiting the risk of incorrect operation (R(λ) = P(execution and error)).
The paper first proves that increasing the stopping threshold does not necessarily reduce this risk, as additional reasoning processes may overturn the initially correct prediction. Theorem 1 decomposes the risk change into transitions from correct to incorrect, from incorrect to correct, and delays in executing the incorrect operation. Subsequently, the author establishes non-identifiability results.
To this end, this paper adopts fixed-sequence LTT, which obtains risk guarantees without monotonicity assumption. Experiments on multi-agent negotiation and single-agent self-correction study the instability of the answer, the non-monotonicity of risk, and the resulting trade-off between automation and risk.
Critical strengths
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This paper uses rigorous probabilistic language to describe a common phenomenon: demanding a higher degree of confidence before taking action may lead to subsequent reasoning overturning the previously correct answer and resulting in worse decisions. The decomposition in Theorem 1 clearly depicts this effect. The non-identifiability construction in Theorem 4 further explains why the overall performance usually fails to reflect the transformation of the underlying correctness. It is meaningful to describe this phenomenon using strict probabilistic language
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The approach proposed by this paper is reasonable, and the theoretical proof seems to be correct (based on my initial assessment). The article also conducted a series of experiments to prove the idea.
Critical weaknesses
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While the studied problem is of interest, much of the formal results follows from relatively elementary probability arguments or already established risk-control framework. The contribution appears primarily interpretive rather than a new statistical framework. Moreover, Theorem 6 is an application of existing fixed-sequence LTT with appropriate sample splitting, as the authors acknowledge. From the perspective of methodology and the depth of theory, the contribution needs to be clarified. More importantly, the paper seems to have failed to adequately discuss the existing literature on early exit under risk control. This largely determines my assignmenton the new contributions made to the article. Specifically, Schuster et al. (Confident adaptive language modeling, NeurIPS 2022) seem have discussed non-monotonic performance as exit thresholds vary and use LTT for PAC calibration. Jazbec et al. (Fast yet Safe: Early-Exiting with Risk Control, NeurIPS 2024) seem have distinguished pointwise loss monotonicity from marginal risk monotonicity and study both expected-risk and high-probability guarantees for sequential exit decisions. Although these papers considered different settings, their concepts and methods seem to have significant overlap with existing work. Therefore, a more detailed comparison is necessary.
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Although the paper shows that stopping risk can be non-monotone, its practical impact seems to be limited. Figure 3 shows that harmful threshold pairs account for at most 1.6% of evaluated pairs, and Appendix K.1 reports a maximum automation loss of only 0.73% from monotone search. Figure 4 primarily demonstrates the known distinction between expected-risk and high-probability guarantees, rather than the benefit of addressing non-monotonicity. Stronger empirical evidence is needed to demonstrate the practical significance of this work.
Questions for authors
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Could the authors clarify the precise theoretical and methodological differences from Schuster et al. (NeurIPS 2022) and Jazbec et al. (NeurIPS 2024)? Can the approach described in the article for handling non-monotonic risks be transferred to some of the existing works, such as Yu et al. (Anytime Safe PAC Efficient Reasoning, ICML 2026)?
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How does the proposed method compare with other high-probability risk-control procedures under the same risk definition? The comparisons in Appendix I are very useful, but they would be even more helpful when compared with more appropriate baselines.
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I read the article very carefully, but to understand it, I had to make guesses based on my domain knowledge. The main thread of the article is mixed with too much supplementary clarifications (maybe you can clarify these issues in the remark or other places), which makes the reading less smooth. There are also some confusing notations in the article, such as the subscript of the probability in equation (6). Making detailed revisions to these issues will significantly enhance the clarity of the article.
I don't mind improving my score if the author can provide reasonable responses to the aforementioned potential weaknesses and questions.
6 comments
W1 (cont.). RELATION TO EARLY EXIT WITH RISK CONTROL
"Insufficient discussion of early exit with risk control (Schuster et al.; Jazbec et al.)."
Related Work (§6) now discusses both papers and Yu et al. (2026), and Appendix B adds the point on Jazbec et al. below. Their relation to ours:
| Prior work | Target | Monotonicity assumed | Relation to this paper |
|---|---|---|---|
| CALM (2022) | Consistency with full model, high-prob. | None (fixed-sequence LTT) | Shared calibration machinery; no identification result |
| Jazbec et al. (2024) | Performance gap; CRC and UCB | Marginally monotone network, hence monotone risk (their Lemma 1) | Prop. 6: marginal risk monotonicity alone does not validate raw CRC for wrong-action risk |
| Yu et al. (2026) | Performance loss, anytime-valid | None needed (anytime-valid sequential testing) | Different feedback model (online, partial) |
The marginal-risk argument of Jazbec et al. The step from their Eq. (14) to the final loss comparison (Appendix A.1) requires additional justification: the augmented-sample threshold depends on the test instance, so its expected population risk and its expected loss on that instance need not coincide.
Pointwise loss monotonicity would establish the required inequality directly, whereas marginal risk monotonicity alone does not; the counterexample in CRC's own Proposition 1 already has a non-increasing risk curve. Proposition 6 makes this distinction precise for wrong-action risk.
Their UCB guarantee is a fixed-sequence test and is unaffected, and we do not claim a failure of their performance-gap guarantees (Appendix B).
W2. PRACTICAL SIGNIFICANCE AND EMPIRICAL EVIDENCE
"Limited practical impact: harmful pairs ≤1.6%, a 0.73 pp search cost; Figure 4 shows a known distinction."
As the reviewer notes, harmful pairs and the measured automation penalty are small. Neither quantity directly establishes whether the pointwise monotonicity assumption required by standard CRC holds. The revision distinguishes them from direct measurements of premise violations and from the statistical consequences of those violations:
| Quantity | Value | What it measures |
|---|---|---|
| Harmful threshold pairs | ≤1.6% (Fig. 3) | Net risk increases; depends on the grid and on the balance of breakage, repair and deferral |
| Premise violations (own loss non-monotone) | 0.54–3.48% of instances; 1.1% → 4.2% with the horizon (§5.1, Table 25) | The assumption standard CRC needs |
| Violations under couplings preserving the evaluated summaries | MMLU-Pro 1.15% → 12.9% (Table 29) | What aggregate summaries cannot detect |
| CRC's expected risk under those couplings | Below in every simulated coupling (Table 29) | Observed size of the effect |
| Prop. 6(i) upper bound on the excess | ≤0.9 pp (10-threshold grid), ≤4.9 pp (paper's grid), | Worst case over compatible couplings, not an observed violation |
| Monotone-search cost | 0.73 pp (App. K.1) | Automation lost on an exactly known curve, not a validity violation |
| Draw-wise exceedance | Plug-in ≤66%, CRC ≤52%, LTT ≤8.5% of draws (Fig. 4a) | Expected-risk versus draw-wise control |
A nearly monotone risk curve is therefore insufficient to settle the premise, and our case rests on the identification and validity results rather than on a large measured automation penalty.
Figure 4 does address a separate question, expected-risk versus draw-wise control, and does not contradict CRC's own expected-risk target; Figure 3 studies structural non-monotonicity, and the revision makes the division explicit.
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Q1. RELATION TO PRIOR WORK AND TRANSFER TO B-PAC
"Differences from Schuster and Jazbec? Transfer to Yu et al.?"
The comparison above identifies the shared tools and the distinct results. B-PAC's validity rests on anytime-valid sequential testing under online partial feedback, not on monotonicity, so Proposition 6 does not show a failure of its guarantee.
Our approach transfers directly to an offline wrong-action evaluation when complete labelled trajectories are available: fix the candidate policies independently of an i.i.d. certification set and apply Corollary 12 (validity for any pre-specified family), with no monotonicity requirement.
With online partial feedback, preserving B-PAC's anytime guarantee would instead require valid policy-specific feedback estimators and sequential tests, which the offline binomial test does not provide. Theorem 1 applies whenever the candidate routing or stopping rules are nested stopping times.
Q2. COMPARISON WITH OTHER HIGH-PROBABILITY PROCEDURES
"Comparison with other high-probability procedures under the same risk?"
The original Appendix I includes Bonferroni LTT, plus singleton-set and stability policies certified by the same fixed-sequence wrapper (Tables 4 and 10); fixed-sequence versus Bonferroni automation is 82.3% versus 77.1% on MMLU-Pro and 82.7% versus 60.0% on BBH.
The revision adds a matched comparison with the same risk, score, grid, budget, calibration draws and untouched deployment set for every selector (Tables 26–27; , 400 draws, ).
Cells show deployment automation / % of draws exceeding :
| Selector | MMLU-Pro | LogiQA | ARC | BBH | MuSR |
|---|---|---|---|---|---|
| Fixed-sequence LTT, exact binomial | 70.1 / 8.5 | 56.5 / 1.2 | 21.4 / 4.0 | 54.1 / 7.0 | 21.9 / 0.0 |
| UCB inversion, Clopper–Pearson | 70.1 / 8.5 | 56.5 / 1.2 | 21.4 / 4.0 | 54.1 / 7.0 | 21.9 / 0.0 |
| Fixed-sequence LTT, Hoeffding–Bentkus | 66.4 / 4.8 | 50.2 / 0.2 | 21.4 / 4.0 | 22.5 / 2.5 | 19.4 / 0.0 |
| Holm, exact binomial | 44.3 / 0.2 | 36.9 / 0.0 | 0.0 / 0.0 | 0.0 / 0.0 | 15.0 / 0.0 |
| Bonferroni, exact binomial | 44.3 / 0.2 | 36.9 / 0.0 | 0.0 / 0.0 | 0.0 / 0.0 | 15.0 / 0.0 |
UCB inversion that scans thresholds cautious-first and stops at the first uncertified one is itself a fixed-sequence test; with an exact Clopper–Pearson bound it coincides with our selector on every draw.
All five procedures are valid under their stated assumptions, and exact fixed-sequence testing ties for the highest automation among those evaluated. This is an empirical comparison, not a universal dominance claim: a fixed sequence can miss safe candidates beyond its first non-rejection.
The gain here comes from an exact test for the binary loss and a pre-specified order with no grid-wide multiplicity penalty.
Q3. CLARITY AND NOTATION
"Clarity; the subscript in Eq. (6)."
Eq. (6) now defines both subscripts as randomness over the certification sample, with score, grid and budget held fixed. We shortened §2 and §5.3 and made the thread explicit:
Mechanism (Thm 1) → Identification (Thm 4) → Consequence for CRC (Prop 6) → Certification (Thm 7)
Remark 1 states exactly where revision enters: without it, the individual loss is monotone automatically.
CONCLUDING REMARKS
Reviewer 8sfJ's questions helped us sharpen both the attribution and the theoretical contribution.
In light of Proposition 6, the matched comparisons and the additional evidence on practical significance, we would appreciate a reassessment of the novelty and significance concerns, and we welcome further discussion of any step.
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We thank Reviewer
8sfJfor the close reading, and for finding the decomposition clear and the non-identifiability construction meaningful. The revision addresses the novelty, significance and baseline questions directly. Changes are in red, and the old Theorem 6 (validity) is now Theorem 7.W1. THEORETICAL NOVELTY AND RELATION TO EXISTING FRAMEWORKS
"Elementary arguments or an existing framework; Theorem 6 applies existing LTT."
The identification problem behind risk-controlled stopping. Each ingredient is familiar: answers flip, CRC needs monotone losses, and CRC can fail when losses are not monotone. The contribution is the distinction between them that is easy to miss, namely that a monotone population risk curve, the quantity one can estimate and check, does not certify the instance-level monotonicity the guarantee requires. That the distinction is subtle is shown by the literature itself: one step of the marginal-risk argument of Jazbec et al. relies on it (W1 cont. below).
The central result is identification. Theorem 4 constructs one set of aggregate summaries (the full risk and automation curves, score-process distribution and all round-wise accuracies) compatible with every pointwise violation rate between 0 and 1. Even exact knowledge of these quantities therefore cannot settle the premise. This is stronger than observing that average monotonicity does not imply individual monotonicity.
Its consequence for CRC (new Proposition 6). In a separate construction, two populations with identical aggregate summaries of the same kind make the same raw CRC selector meet its expected-risk target on one and violate it on the other. With w=⌊ε(n+1)⌋−1 and π=Pr(Bin(n,p)≤w)>0, the two expected risks are
pπ≤ε,p1−(1−π)T,
the second exceeding ε exactly when
T>log(1−π)log(1−ε/p).
These are theoretical constructions, not violations observed in LLM data.
Attribution. The independent-loss population P1 is the counterexample in the proof of CRC's Proposition 1 (Angelopoulos et al., 2024), also analysed by Aldirawi et al. (2026); the revision credits Angelopoulos et al. in §3 and both in Appendix A.
Our additions are a valid population P0 with the same aggregate summaries, and a curve-dependent upper bound on the excess for every coupling:
E[R(λ^CRC)]≤ε+Δn(R),
\Delta_n(R)=\int_\varepsilon^1\min\left\\{1,\sum_{j:\\,R(\lambda_j) > r}F_{R(\lambda_j)}\right\\}\\,dr,
with
Fr=Pr(Bin(n,r)≤⌊ε(n+1)⌋−1).
Part (ii) concerns CRC on the raw loss; the loss-monotonised variant of Angelopoulos et al. is valid by construction, at a cost in automation (Appendix A).
From selection bias to non-identifiability. In P0 each instance is right at every round or wrong at every round, so the calibration error counts at the acting thresholds move together. In P1 correctness is redrawn each round, so the counts vary independently, and CRC, which selects the least cautious passing threshold, can select an over-budget threshold that passes by chance.
The mechanism is a selection effect; what is new is that the dependence driving it is not identified by the summaries above, so they cannot, in general, determine whether CRC meets its target. Proposition 6(i) bounds the possible cost, with equality approached by this family as the horizon grows; we do not claim finite-horizon sharpness.
The results form one chain:
The probabilistic arguments are relatively simple; their contribution is the identification result they establish. We claim no novelty for fixed-sequence LTT: Theorem 7 states the independence conditions under which it certifies our fitted stopping policies.
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