acceptodds
Under review as a conference paper at ICLR 2027

SteadyStop: Risk-Aware Early Stopping for Efficient Reasoning

Abstract

Long chains of thought can improve problem solving, but models may continue generating after a useful answer is already available. Stopping earlier can reduce this redundancy, yet an interruption may discard reasoning needed to reach a correct answer. Efficient stopping therefore requires distinguishing readiness to answer from the risk of interrupting an otherwise successful trajectory. To address this problem, we propose SteadyStop, a lightweight stopping framework with separately learned Readiness and Hazard signals. Readiness is trained to predict whether all sampled early answers are correct, while Hazard targets unreliable early answering when full reasoning produces a correct answer. Both signals are learned from reference-checked outputs of the same model using two linear heads with 66 trainable parameters. A Steadiness condition reuses Readiness from the preceding anchor, and the first passing anchor triggers one final answer. The reasoning model remains unchanged, with no auxiliary language model required for annotation or online verification. Across two reasoning models and three mathematical benchmarks, SteadyStop reduces output length by 22.86% with a 0.21 percentage point decrease in accuracy, averaged equally over the six settings. This yields a larger mean token reduction and a smaller mean accuracy decrease than the four evaluated baselines.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Overthinking, Early Stop, Efficient Reasoning

Reviews

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1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
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Paper summary

This paper aims to develop an early stopping for reasoning models. To this end, the paper first introduces three signals: readiness, hazard, and steadiness. Then, the authors propose training a classifier that gets hidden states at specific parts of reasoning called “anchors" and predicts readiness and hazard signals. At inference time then, the model stops reasoning if readiness and steadiness are larger than their corresponding thresholds and hazard is lower than its threshold. Across two reasoning models and three math datasets, the authors showed that their proposed model outperforms some but a limited number of baselines.

Critical strengths

I think introducing the readiness signal is the main strength of the paper. However, lack of more analysis and sufficient ablation for it makes it hard to understand the effect of these.

Critical weaknesses
  1. The comparisons are generally limited in datasets, models, and baselines. The authors could strength their results by adding at least the AIME dataset, another non Qwen model, and baselines such as RCPD[1], CoDE-Stop[2], and On-policy SFT [3]. As of now, the results are very limited.

  2. I think this paper is heavily suffering from not having a strong motivation and ablation behind its method. The authors mentioned that they have used the last 3 anchors to get the signals. Why not 2 or 5? Or why should the steadiness signal work? what is the motivation behind it? These are interesting engineering techniques but without much justification.

[1] Hosseini, Parsa, et al. "Early Stopping for Large Reasoning Models via Confidence Dynamics." arXiv preprint arXiv:2604.04930 (2026).

[2] Wang, Xi, et al. "Conformal thinking: Risk control for reasoning on a compute budget." arXiv preprint arXiv:2602.03814 (2026).

[3] Zhao, Anhao, et al. "On-policy supervised fine-tuning for efficient reasoning." arXiv preprint arXiv:2602.13407 (2026).

Questions for authors
  1. Please take a look at the weaknesses.

  2. The reported Acc of DEER on DeepSeek-R1-Distill-Qwen-7B and GSM8k has been around 90% [1]. However, the reported Acc for DEER on DeepSeek-R1-Distill-Qwen-14B in the paper is around 80%. What is the setup and hyperparam used for DEER?

  3. Could the authors add the baselines to Table 3. Right now it doesn't convey much information about the transfer capabilities. Also, I am curious about transfer to AIME because it generally requires more reasoning budgets.

[1] Zhao, Anhao, et al. "On-policy supervised fine-tuning for efficient reasoning." arXiv preprint arXiv:2602.13407 (2026).

4 comments

W1

Short answer: We have added a non-Qwen model (DeepSeek-R1-Distill-Llama-8B, four benchmarks) and AIME 2024/2025 (all three models). Of the three suggested baselines, Conformal Thinking releases no runnable code. On-policy SFT trains the target model, whereas our method leaves the target model untouched. CoDE-Stop scores answers with a GPT-4o-mini judge, but our method relies on no external model at any stage, since the labels come from the target model's own rollouts and answers are checked by symbolic equivalence. We consider our method a clear advance over the last two approaches, so we do not present these three as aligned comparisons, and our primary comparison set remains the methods in Table 1.

Added model and data.

See Table R3 in our response to Reviewer APpp, W2 & Q2.

The same trade-off is reproduced on a non-Qwen architecture, which indicates that the signals are not specific to the Qwen family.

See Table R4 in our response to Reviewer APpp, W2 & Q2.

On AIME, the controller removes 14.8–25.0 % of tokens and loses 1.67–3.33 pp. The reduction is smaller than on GSM8K or MATH-500, which is expected: harder problems determine their answer later, so fewer tokens can be removed safely.

Following the references in the review: [1] is CoDE-Stop (arXiv:2604.04930), [2] is Conformal Thinking (arXiv:2602.03814) and [3] is On-policy SFT (arXiv:2602.13407).

CoDE-Stop (arXiv:2604.04930) scores each candidate answer with a GPT-4o-mini judge and generates a trial answer at every reasoning step, so its per-query cost grows with the length of the trace. Our controller needs neither: it reads one hidden state and applies two linear heads with 66 parameters, which costs 0.2–4.5 ms per query.

For Conformal Thinking (arXiv:2602.03814, ICML 2026), the code is not publicly available for this work, so we are unable to reproduce its results.

On-policy SFT (arXiv:2602.13407) requires training a model: it needs a data pipeline, a filtering or reward design, a training run, and the result is a new checkpoint. SteadyStop does not train models: it reads hidden states at inference and applies two linear heads with 66 parameters. This keeps the base checkpoint intact, needs no training infrastructure and applies to frozen models, which is a clear step forward over the training-based recipe.

Both CoDE-Stop (arXiv:2604.04930) and On-policy SFT (arXiv:2602.13407) are preprints without a peer-reviewed version at the time of writing, so we did not adopt them as the primary comparison set; our primary baselines are the peer-reviewed methods with released code in Table 1, all run under identical protocols.

Takeaway. The revised paper now covers a non-Qwen model and a harder benchmark, and all three suggested baselines are addressed with explicit reasons rather than silently omitted. The training-free, judge-free design of our controller is stated as a clear advantage over the alternatives.


W2

First, a clarification. The method does not use the last three anchors. In §3.2 and Figure 2, "three early answers per anchor" refers to performing three truncations at each anchor and collecting the corresponding answers, and they are used to construct the Readiness label (an anchor is labelled ready if all three truncated answers are correct).

Most early-stopping methods in this literature rely on the model's internal confidence — how sure it is of the answer it is about to give, or whether it can already produce a correct answer at this point. Readiness implements exactly that signal. It is necessary but not sufficient, for two reasons we observed while building the training data:

A confident stop can destroy an answer that was going to be right. At many anchors, the model can still reach the correct answer if it keeps going. However, if the model answers immediately with only a short prompt-forced finalization, it may produce a wrong answer. Confidence-based gating cannot see this case, because the signal is computed from the partial reasoning rather than from what the forced answer would actually be. Hazard detects precisely this event: it is trained on "the full trajectory is correct but early answering is not".

Readiness jumps. We observed discontinuous jumps in Readiness from one anchor to the next, when the model switches strategy, guesses, or has an "aha moment". Such a jump is sometimes good for solving the problem, but is not a reliable stopping target, because the jump happens when the model finishes a sub-goal of the reasoning, not when the model is able to solve the problem as a whole. A threshold on a single anchor can fire at the jump, and the controller then stops before the remaining reasoning is produced, leading to an incorrect final answer. Steadiness addresses this by requiring the previous anchor's Readiness to also exceed a threshold.

Why one preceding anchor, and not two or five. A lag of one is the minimal confirmation that removes single-anchor spikes, adds no parameter and no extra head, and preserves the earliest safe stopping point. A longer lag delays every stop by at least one anchor and reduces the token saving, without contributing information that the Readiness heads do not already encode.

The ablation supports this reading. Removing one gate condition at a time while keeping the fitted heads and thresholds (Table 2) gives:

ConfigurationGSM8KMATH-500AMC
SteadyStop84.84 / 113780.80 / 311065.06 / 6671
Without Steadiness80.14 / 78774.00 / 217353.01 / 4211
Δ accuracy−4.70 pp−6.80 pp−12.05 pp

Removing Steadiness makes the gate more permissive and the token count collapses. The accuracy loss (4.70 to 12.05 pp) is far larger than threshold variation alone would produce.

Takeaway. The three signals are not arbitrary additions: each is motivated by observed failures of the prior design, the lag and the number of early answers are deliberately minimal rather than tuned, and the ablation quantifies the contribution of each signal.


Q2

Short answer: The two figures are produced under different protocols and different basic setups, so they are not directly comparable. Moreover, when we raise the budget substantially, our 14B GSM8K accuracy rises to a normal, competitive level, which confirms that the earlier figure reflects the budget rather than the model.

Experimental infrastructure, decoding parameters, and generation budgets vary across different papers. Experimental data reported for a baseline in one paper are measured under its protocol, and comparing it with data measured on ours mixes two different measurements. This is why we do not compare against numbers reported elsewhere at all, and every entry in Table 1 is produced by us under a single protocol and a single setup.

The 14B model is substantially stronger than the smaller checkpoints used in several baselines, so we think a large generation budget is not needed for it to reach a stable answer. We use 4,096 tokens for GSM8K, 8,192 for MATH-500, and 10,240 for AMC. The fraction of traces that exhaust the budget is correspondingly small, so the differences between methods reflect their stopping behaviour rather than truncation.

Excerpted from Table 1 (GSM8K, 14B, mean of three runs):

MethodAcc.↑Tokens↓
Full reasoning83.90804.82
TokenSkip84.05719.46
SBT-D83.24696.83
DEER83.47702.84
T-Calibration83.67748.27
SteadyStop (ours)85.97677.57

Our method has both the highest accuracy and the fewest tokens at this setting, which is the comparison the paper actually claims.

With a 16,384-token budget, the 14B model reaches a normal accuracy level:

GSM8K, DeepSeek-R1-Distill-Qwen-14B @ 16,384Acc.↑Tokens↓
Full reasoning92.49868.2
SteadyStop91.13706.9

Raising the budget moves full reasoning from 83.90 % to 92.49 %, and it is close to the 93.9 % that DEER reports for this checkpoint at 16,384 tokens. Also, at the larger budget, the controller no longer gains accuracy: it removes 18.6 % of the tokens at a cost of 1.36 pp. The positive gap in Table 1 is therefore specific to the smaller budget, where part of full reasoning's output consists of traces that reach the cap without a usable answer.

DEER is run under exactly the same settings as our main experiment — the same prompts, the same 4,096 / 8,192 / 10,240 budgets and the same decoding parameters — so every number in Table 1 comes from a single protocol.

Takeaway. The apparent gap is explained by differences in protocol and basic setup rather than by an unfair comparison, and under a strictly shared budget and decoding configuration our method is favourable against every compared baseline.


Q3

We thank the reviewer for both suggestions.

Due to time and compute constraints, we have not yet finished the relevant experiments, and these runs will be added in the follow-up experiments. For the AIME extension, we refer the reviewer to the AIME section of our responses to W1, where the added benchmark and its generation budget are described.

I appreciate the authors for providing more experimental results, but my main concerns mostly remain.

W1.

I think the paper needs a comparison with methods that already show improvements over DEER. For example, this can be Conformal Thinking if the authors reimplement their method, or CoDE-Stop and On-policy SFT.

W2.

Thank you for the clarification about this. I misinterpreted this part from the paper. However, I still think the supporting evidence and analysis for why these new signals work is limited.

Q2.

Thanks for providing the explanation. This resolves my issue.

Q3.

I appreciate the new experiments. However, again, without having other baselines on AIME, I am not sure how informative the results are.

In general, I still think some baselines stronger than DEER are missing and the method lacks deeper analysis. Therefore, I will maintain my score.

Reviewer_APppOpenReview ↗
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Paper summary

SteadyStop addresses the trade-off between reducing redundant reasoning and interrupting trajectories that would eventually produce a correct answer. It trains two linear heads on hidden states of a frozen reasoner: Readiness predicts whether three sampled early answers are all correct, while Hazard predicts unreliable early answering when the complete trajectory succeeds. A persistence condition reuses the preceding anchor's Readiness score. Thresholds are selected on a held-out calibration split, and the first anchor satisfying all three conditions triggers a final answer. Across two backbones and three mathematical benchmarks, the paper reports a 22.86% mean reduction in returned output length with a 0.21-percentage-point macro-average accuracy decrease.

Critical strengths
  1. The paper formulates early stopping as a risk-aware decision, separating answer readiness from the risk of premature termination. Hazard uses both early-answer outcomes and full-trajectory correctness, and Steadiness adds temporal consistency.

  2. The method is lightweight and easy to implement: two linear heads with 66 parameters, no modification to the reasoning model, no auxiliary language model, and no additional trial answers at inference.

Critical weaknesses
  1. The paper's main claim is that the separately trained Hazard head adds value beyond Readiness, but this is not established. Section 3.3 defines the labels so that ℓR + ℓH ≤ 1, and removing Hazard improves both accuracy and token efficiency on AMC. Table 2 also removes gates while retaining the fitted heads and prefix features, so it does not isolate recalibration; matched-token-budget comparisons are needed.

  2. The feature design and generalization are under-validated. The choice of PCA to 32 dimensions is not justified, and there is no comparison with raw hidden states, other dimensions, or alternative projections; the hidden-state difference term is also not ablated. Both models are Qwen-based and the main tasks are mathematical, including the relatively simple GSM8K; the CommonsenseQA and ARC-Challenge transfer provides only limited evidence.

  3. Efficiency is measured only by token counts. The paper does not report latency, throughput, or end-to-end cost, and the offline cost of sampling multiple early answers at every anchor is not quantified.

Questions for authors
  1. What does Hazard capture beyond Readiness given the Section 3.3 constraint ℓR + ℓH ≤ 1? Please compare against a Readiness-only controller with independently recalibrated thresholds and matched token budgets; this would also clarify whether the ablation comparisons are fair.

  2. Can you justify PCA-32 with ablations using raw hidden states, other projection dimensions, alternative dimensionality reduction methods, and the hidden-state difference term? Can you also evaluate non-Qwen models such as Llama or Gemma and more challenging tasks beyond math and multiple choice?

  3. Can you report wall-clock latency, throughput, and end-to-end cost, and quantify the offline data-collection cost of generating three early-answer samples per anchor?

3 comments

W1 & Q1

We changed the ablation design, and we trained a Readiness-only controller and recalibrated its thresholds independently. That controller loses accuracy on all three benchmarks (−0.61, −1.60, −2.41 pp) and uses more tokens on GSM8K and MATH-500.

Hazard targets one specific failure: the model can solve the problem correctly in the untruncated setting, but makes an error due to premature termination at a certain reasoning step. Readiness labels the anchors with a wrong early answer negative as well, but it cannot tell whether the full trajectory would have been correct. Hazard supplies exactly that information, so the two labels are mutually exclusive (ℓR + ℓH ≤ 1) but not redundant: ℓH = 1 only for the anchors whose trajectory would have ended correctly. How the new ablation is built. It keeps only the Readiness head, and its thresholds are selected independently on the calibration set.

BenchmarkDifficultySteadyStop Acc.↑SteadyStop Tokens↓Readiness-only Acc.↑Readiness-only Tokens↓Δacc
GSM8Keasy84.84 %1137.184.23 %1228.8+0.61 pp
MATH-500medium80.80 %3110.379.20 %3132.5+1.60 pp
AMChard65.06 %6671.562.65 %6441.6+2.41 pp

Removing Hazard lowers accuracy on all three benchmarks, and the loss grows with difficulty (0.61 → 1.60 → 2.41 pp). This is consistent with the mechanism above: the harder the problem, the more often a nearly sufficient prefix is reached, and the more costly it is to stop prematurely. Hazard can also bring a small negative effect. On AMC, the full controller spends 230 more tokens (6,671 vs 6,442, +3.6 %), because it may block a prefix that would in fact have been safe; on GSM8K and MATH-500 the same condition reduces tokens instead (1,137 vs 1,229 and 3,110 vs 3,133). The benefit therefore dominates the cost. Both controllers are calibrated under the same accuracy constraint (drop ≤ 2 pp) and both metrics are reported, so the trade-off is visible: the full controller is more accurate on all three benchmarks and cheaper on two of them. In summary, Hazard separates anchors that Readiness cannot separate, and the recalibrated ablation now supports it.


W2 & Q2

Short answer: The encoding was fixed a priori and was never tuned on any evaluation set. The more substantive gap was coverage, so we added two experiments: a non-Qwen model, DeepSeek-R1-Distill-Llama-8B, and AIME 2024/2025 on all three models.

We fixed the encoding once (PCA to 32 dimensions on the concatenation of h_{n(k)} and h_{n(k)} − h_{n(k−1)}) and kept it for all models and benchmarks. A per-benchmark projection would turn an implementation detail into an implicit hyperparameter, and it would make the baseline comparison less clean. The two heads are linear layers with 66 parameters in total. Fixed, untuned PCA follows existing practice: Thought calibration (Wu et al., EMNLP 2025)[1] applies PCA to 256 dimensions without an ablation. We therefore keep the encoding fixed rather than tuned, and we agree that an encoding ablation would strengthen the paper. If sufficient time and compute resources become available, we will add it in the revision.

[1] Wu, Menghua, et al. "Thought calibration: Efficient and confident test-time scaling." In Proceedings of EMNLP (2025), pp. 14291–14305. We added a non-Qwen model, DeepSeek-R1-Distill-Llama-8B, using the same controller and the same calibration procedure:

Table R3 — Non-Qwen model (DeepSeek-R1-Distill-Llama-8B).

ModelBenchmarkRaw (Acc / Tok)SteadyStop (Acc / Tok)ΔaccRed.↑
DeepSeek-R1-Distill-Llama-8BGSM8K90.14 / 1470.189.08 / 1099.4−1.06 pp25.2
MATH-50080.60 / 3930.483.40 / 3125.3+2.80 pp20.5
AMC79.52 / 6684.877.11 / 5318.4−2.41 pp20.4
AIME 24/2541.67 / 14903.338.33 / 11181.2−3.33 pp25.0

The same trade-off is reproduced on a non-Qwen architecture, which indicates that the signals are not specific to the Qwen family. We also extended the evaluation to AIME 2024/2025 (60 questions). Table R4 — AIME 2024/2025.

ModelMethodCorrect/60Tokens↓Red.↑
Qwen3-1.7BFull reasoning23/6017425.9–
SteadyStop21/6014559.216.4
DeepSeek-R1-Distill-Qwen-14BFull reasoning39/6011132.6–
SteadyStop38/609484.914.8
DeepSeek-R1-Distill-Llama-8BFull reasoning25/6014903.3–
SteadyStop23/6011181.225.0

On AIME, the controller removes 14.8–25.0 % of tokens and loses 1.67–3.33 pp. The hidden-state encoding is an implementation choice rather than a tuned core parameter. We also added a non-Qwen model and a harder benchmark to address the coverage concern.

W3 & Q3

Short answer: Latency falls by 19.7–30.5 % and questions per minute rise by 25–39 % on all six pairs, and the controller adds less than 0.25 % latency overhead. The offline labelling pass costs 12.7 M tokens (1.7B) or 7.5 M (14B) per 1,000 questions, and it is paid once per model.

Measurements use batch size 1 on the same GPU with identical prompts and budgets; throughput is reported in tokens/s and in completed questions per minute.

See Table R1 in our response to Reviewer hxEG, W1.

What the numbers show. Latency falls on all six pairs. The gain is largest on AMC with 14B (339.36 s → 235.93 s), because longer traces benefit more from truncation. Decode speed does not change (21.6–27.2 tok/s), so the saving comes from fewer generated tokens. The single drop (GSM8K, 1.7B: 26.9 → 21.7 tok/s) comes from a fixed overhead in every request, so we also report questions per minute (0.87 → 1.19).

The controller overhead is negligible, and a single probe costs:

See Table R2 in our response to Reviewer hxEG, W1.

Each anchor needs three 16-token early answers; the table below accounts for one question, and the total assumes the 1,000-question calibration set we used.

ComponentQwen3-1.7BDeepSeek-R1-Distill-Qwen-14B
Anchors per question (mean)136.076.5
Prompt~400~400
Full reasoning trace (mean)3,0201,902
3 early answers per anchor (16 tokens each)6,5283,672
Cue segments per question2,7201,530
Total per question~12,668~7,504
Total for 1,000 questions~12.7 M~7.5 M

Labels, heads, and thresholds are computed once and reused for every benchmark and ablation. The pass is embarrassingly parallel, and each early answer is capped at 16 tokens, so the cost does not grow with the deployment budget.

The efficiency claim is now supported by wall-clock measurement rather than token counts alone, and the labelling cost is quantified, one-off, parallel, and smaller in kind than the training cost of model-adapting alternatives.

Reviewer_hxEGOpenReview ↗
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Paper summary

This paper proposes SteadyStop, a lightweight early-stopping framework for efficient reasoning. The key idea is to distinguish Readiness, which estimates whether the current reasoning prefix is sufficient for answering, from Hazard, which estimates the risk of interrupting a trajectory that would otherwise reach a correct answer. A Steadiness condition further requires consistent evidence across consecutive anchors. The method keeps the reasoning model frozen and uses only two linear heads. Experiments on two reasoning models and three mathematical benchmarks show an average token reduction of 22.86% with only a 0.21 percentage-point accuracy decrease.

Critical strengths
  1. The paper addresses a clear and practically important problem: long reasoning trajectories often contain substantial redundant computation.
  2. The distinction between readiness to answer and the risk of harmful interruption is well motivated and directly addresses the limitation of using a single stopping confidence signal.
  3. The method is lightweight and does not require updating the underlying reasoning model or using an auxiliary LLM during inference.
  4. The empirical results are convincing: SteadyStop achieves substantial token reduction while largely preserving accuracy, and compares favorably with the evaluated baselines.
  5. The ablation results generally support the roles of Readiness, Hazard, and Steadiness.
Critical weaknesses
  1. The paper mainly evaluates efficiency through generated token count. Additional wall-clock latency or throughput results would make the practical efficiency claim stronger.
  2. These experiments still cover a relatively limited range of reasoning behaviors. It remains unclear how reliably the stopping signals would transfer to domains with substantially different reasoning structures, such as coding, scientific reasoning, long-horizon planning, or tool-augmented reasoning.
Questions for authors

see weaknesses

1 comment

Weakness1

We thank the reviewer for pointing out that token counts alone do not reflect deployment cost. We have added wall-clock latency and throughput measurements.

Short answer: SteadyStop reduces end-to-end latency by 19.7–30.5 % and raises throughput by 25–39 %, while the controller adds less than 0.25 % overhead.

Table R1

ModelBenchmarkMethodLatency↓ (s)Thru.↑ (tok/s)Q/min↑
Qwen3-1.7BGSM8KFull reasoning69.0826.90.87
SteadyStop50.2721.71.19
MATH-500Full reasoning160.7426.30.37
SteadyStop124.1425.30.48
AMCFull reasoning324.5527.20.18
SteadyStop243.4027.20.25
DeepSeek-R1-Distill-Qwen-14BGSM8KFull reasoning41.5722.81.44
SteadyStop33.3922.81.80
MATH-500Full reasoning150.0922.40.40
SteadyStop116.1722.50.52
AMCFull reasoning339.3621.60.18
SteadyStop235.9321.80.25

What the numbers show. Latency falls on all six pairs. The gain is largest on AMC with 14B (339.36 s → 235.93 s), because longer traces benefit more from truncation. Decode speed does not change (21.6–27.2 tok/s), so the saving comes from fewer generated tokens. The single drop (GSM8K, 1.7B: 26.9 → 21.7 tok/s) comes from a fixed overhead in every request, so we also report questions per minute (0.87 → 1.19).

The controller overhead is negligible, and a single probe costs:

Table R2

ModelRead hiddenScore + cmpFull probePer queryShare
Qwen3-1.7B0.0781 ms0.1375 ms0.2156 ms3.67 ms0.002–0.007 %
DeepSeek-R1-Distill-Qwen-14B0.1509 ms4.3527 ms4.5036 ms76.6 ms0.032–0.23 %

Takeaway. The speed-up is a real wall-clock effect, and the decision cost is negligible.


Weakness2

We thank the reviewer for raising this. We agree that the scope of early stopping should be stated explicitly, and we address each of the four domains below.

DomainApplicable?Reason
CodingNoPartial code does not compile, so a truncated suffix cannot be reused
Long-horizon planningNoEach step mutates external state, so truncation is irreversible
Tool-augmented reasoningNoLater calls depend on state produced by earlier ones
Scientific reasoningYesThe answer can be produced from an accumulated derivation

Early stopping is valid only when the final answer can be produced from a prefix of the reasoning. These three domains violate that condition, so truncation destroys information that later steps depend on. Scientific reasoning satisfies the condition. But due to time and compute constraints, we have not yet finished the relevant experiments. We will add it with a controller recalibrated on that domain in the final version.

Takeaway. Our method is scoped to prefix-recoverable reasoning, and this boundary is now explicit.


From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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