acceptodds
Desk rejected at ICLR 2027

SabreAgent: Language Models at Design Time for Lost-Sales Inventory Control

Desk rejected at ICLR 2027, so left out of the paper lists and the map.

Abstract

SabreAgent uses a language model at design time to construct two components for lost-sales inventory control: a product-specific seasonal prior and a validation-selected capped base-stock policy family. During operation, statistical forecasting and inventory optimization use these frozen artifacts to determine orders, with zero language-model calls. We evaluate the approach on the instances of InventoryBench. Under the benchmark's cost assumptions, the operations-research core draws on a zero-lead-time optimality result and a projected-inventory rule for positive deterministic lead times. The latter computes replenishment shortfalls by propagating inventory using sales along simulated demand paths. The seasonal prior adds forecast variants alongside the original forecaster, and the selected policy family handles stochastic lead times with order destruction. SabreAgent scores , compared with for the strongest published baseline, and ranks first in all six benchmark cells. Ablations attribute most of the gain to the OR core. In the paired analysis, the seasonal component adds across the three real-data cells, and the search component adds across the two stochastic-lead-time cells. These results demonstrate how model-generated priors and policy structure can improve an OR controller through design-time use.

Primary area:
learning on time series and dynamical systems
Keywords:
Inventory Control, Agent, Large Language Models

Reviews

Among:
Shape:
1234this paper, Bottom 10%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_fzhxOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

The paper proposes SabreAgent, a framework for lost-sales inventory control that uses an LLM during design time rather than in the runtime decision loop. The motivation is that inventory decisions are consequential, and repeatedly asking an LLM to choose orders can be less reliable and more expensive than using a structured forecasting and optimization pipeline. SabreAgent combines three main components:

  • An operations-research control core. For zero lead time, the authors establish a structural result supporting a myopic critical-fractile policy under stationary demand and the benchmark’s cost assumptions. For positive deterministic lead times, they introduce a projected-inventory surrogate that simulates inventory and lost sales along sampled demand paths to estimate replenishment shortfalls.
  • A language-model-generated seasonal prior. The LLM extracts a normalized 52-week seasonal profile from product descriptions. The system combines deseasonalized forecasting variants with the original, unadjusted forecaster, using discounted Bayesian model averaging to adapt their weights online.
  • Automated policy-family selection. An LLM-guided research loop proposes policy changes evaluated on separately generated validation instances. It selects a capped base-stock policy for stochastic lead times, intended to prevent excessively large catch-up orders after order destruction. The policy parameters are subsequently optimized online without LLM calls. The evaluation covers all 1,320 instances of InventoryBench, spanning synthetic and real data under zero, deterministic positive, and stochastic lead times. The reported overall normalized reward is 0.6311, compared with 0.5380 for the strongest published baseline. SabreAgent ranks first in all six benchmark cells. However, the paper’s own ablations indicate that most of the improvement comes from the OR core, which scores 0.6180 on the authors’ batched ablation evaluation path. The model-authored seasonal and policy-search components contribute an additional 0.0138 on that path. The seasonal component improves the real-data cells, while the policy-search component primarily improves the stochastic-lead-time cells. The central contribution is therefore a hybrid design methodology: use an LLM to propose useful priors and policy structures, but rely on explicit cost modeling, statistical forecasting, numerical optimization, and validation to make operational decisions.
Critical strengths

Strength 1 — A compelling separation between design-time intelligence and runtime control

The paper presents a practical architecture in which LLM-generated artifacts are frozen before deployment and runtime decisions are made without language-model calls. This avoids repeated inference costs and reduces dependence on unconstrained model-generated actions. The approach also makes the system more auditable: the seasonal prior, forecasting mixture, control objective, and replenishment rules can be inspected and evaluated separately. This is a meaningful design principle for decision-making systems where actions have economic consequences.

Strength 2 — Strong benchmark performance with useful component-level analysis

The reported improvement from 0.5380 to 0.6311 over the strongest published baseline is substantial, and the method leads across all six benchmark cells. The authors also provide a more informative analysis than a headline score alone: they compare against hindsight diagnostics, report cell-wise results, and conduct component ablations with paired bootstrap intervals. The ablations clarify the source of the gains rather than attributing the entire improvement to the LLM. In particular, the seasonal prior adds value on real-data cells, and policy-family selection improves stochastic-supply settings. This decomposition strengthens the empirical narrative, even though it also narrows the claim about the LLM’s contribution.

Strength 3 — Careful modeling of lost sales and supply uncertainty

The paper explicitly accounts for the benchmark’s unusual but important cost structure: free replenishment, zero salvage value, uncensored demand observations, and possible order destruction. The distinction between inventory position and projected inventory is particularly relevant because lost demand does not deplete stock.The authors also state the scope of their theoretical results rather than claiming general optimality. The zero-lead-time result has explicit assumptions, while the positive deterministic lead-time controller is presented as a surrogate. For stochastic lead times, shared rollout trajectories help reduce variance when comparing candidate policies. These details make the technical approach more principled than simply prompting an LLM to produce orders.

Critical weaknesses

Weakness 1 — Test-informed development weakens the independence of the headline result

This is the most important concern in my assessment. The paper explicitly acknowledges two channels through which test information influenced development:

  • The functional form of the depletion multiplier κ\kappa was chosen after observing a systematic mismatch at the cell level, with coefficients subsequently fitted on validation data.
  • The automated policy-search proposer received four aggregate test diagnostics indicating that stochastic supply was a weak regime.

The authors state that candidate policies were accepted or rejected using validation scores, not individual test scores. This is a meaningful safeguard, but it does not entirely eliminate the concern: the final method and search priorities were informed by test-set diagnostics. Consequently, the 1,320-instance evaluation is not a fully untouched assessment of a development process independent of test feedback. This does not establish that the reported improvement is invalid, but it makes the generalization evidence less convincing than the headline comparison alone suggests. A fresh benchmark or independently held-out test set would substantially strengthen the paper.

Weakness 2 — The LLM-specific contribution is relatively modest and the novelty boundary needs clarification

The frozen OR core already achieves 0.6180 on the batched ablation path, compared with an overall score of 0.6311 for the submitted system on the official evaluation path. The authors report a combined model-authored-component gain of 0.0138 on the batched path. This suggests that much of the performance improvement comes from exploiting the benchmark’s cost structure and implementing a better inventory controller, rather than from LLM-based design itself. Moreover, the selected capped base-stock policy belongs to an established family, and the seasonal component builds on familiar forecasting and model-averaging techniques. The paper does provide technical contributions in projected-inventory control and the integration of design-time artifacts, but it would benefit from a sharper distinction between:

  • Novel theoretical or algorithmic contributions.
  • The application of established OR methods to this benchmark.
  • Improvements specifically attributable to the LLM.

The relevant question is not whether the complete system performs well (it does in the reported benchmark) but whether the paper sufficiently establishes a novel and generalizable contribution to LLM-based algorithm design.

Weakness 3 — External validity is limited by the benchmark and its cost assumptions

The approach is evaluated on one benchmark with a particular operational structure: zero purchase and setup costs, zero salvage value, uncensored demand observations, a short initial history, and a fixed set of supply dynamics. These assumptions are central to the method. In particular, the zero-lead-time theoretical result depends on the cost structure, while the positive-lead-time controller uses a surrogate objective rather than a general optimality guarantee. The paper itself acknowledges that positive purchase or setup costs change the value of carried inventory. As a result, the experiments do not establish that the method will perform similarly in settings with purchase costs, replenishment constraints, censored demand, different lead-time distributions, or different product calendars. The seasonal prior is also evaluated on the real-data portion of this particular benchmark, rather than across multiple independent retail datasets. This is primarily a limitation of the scope of the claims, not necessarily a flaw in the implementation. The paper would be stronger if it either narrowed its claims explicitly or demonstrated robustness under materially different inventory regimes.

Weakness 4 — Evidence for the individual LLM components and online alternatives remains incomplete

The ablations are helpful, but several aspects deserve further scrutiny. First, the policy-search component is credited with improvements in the stochastic-lead-time cells, yet only one of 52 proposed candidates contributes to the final search component. This is compatible with successful automated search, but it leaves open how robust the discovery is to different validation seeds, search budgets, or initial policy families. Second, the seasonal prior is generated using a system prompt that includes manually written priors, category-level seasonal peaks, and retail-calendar information. The observed gain therefore cannot be attributed exclusively to the LLM’s knowledge of product descriptions. A direct comparison against a non-LLM seasonal prior using the same contextual information would help isolate the LLM’s incremental value. Third, the same-model online-adjustment control is evaluated on only 124 instances. Its reported improvements are heterogeneous: all four deterministic-cell estimates are negative, while the real stochastic cell is the only cell with a positive estimate exceeding two standard errors. This is useful preliminary evidence, but it does not support a broad conclusion that design-time use is universally preferable to runtime adjustment. These gaps are particularly relevant if the paper’s primary contribution is intended to be a general methodology for using LLMs to design decision-making systems.

Questions for authors

Q1. Test independence and generalization. Given that the depletion-multiplier functional form was chosen after inspecting cell-level test diagnostics, and that aggregate test diagnostics informed the automated search priorities, how much might these choices have influenced the reported result? Can the authors evaluate the frozen method on a genuinely untouched set of instances or a second benchmark?

Q2. Isolating the contribution of the LLM. Can the authors compare the LLM-generated seasonal prior against a non-LLM baseline that uses the same product descriptions, category-level seasonal information, and retail calendar? How much of the reported seasonal gain comes from the product-specific LLM output rather than the manually supplied priors?

Q3. Robustness of automated policy discovery. How sensitive is the selected capped base-stock family to the validation-instance distribution, random seed, initial policy family, and search budget? Would repeated independent discovery runs select the same family or achieve comparable improvements on an untouched evaluation set?

Q4. Generalization beyond the benchmark. How does the method behave when key assumptions change—for example, when purchase or setup costs are nonzero, demand is censored by stockouts, or lead-time distributions differ from the benchmark’s fixed regimes? Which parts of the theoretical analysis and implementation would need to change in these settings?

1 comment

As there were no responses, I will keep my scores.

Reviewer_czB7OpenReview ↗
Rating
2
Confidence
2
Informativeness
1
Presentation
1
Soundness
1
Read review
Paper summary

The paper introduces SabreAgent, which employs an LLM to offline generate priors for seasonal demand and to search for inventory control strategies, while relying on traditional forecasting and operations research (OR) optimization for online execution. SabreAgent outperforms existing baselines on the InventoryBench benchmark; however, the vast majority of this performance gain stems from the manually designed OR algorithms. The contribution of the LLM is limited, and the study fails to demonstrate that the LLM is indispensable.

Critical strengths
  1. The authors conducted evaluations using 1,320 instances from InventoryBench across six different settings, achieving results that outperform existing baselines.
Critical weaknesses
  1. The motivation for this paper is insufficient. The authors fail to explain why an LLM is indispensable. In the paper, the LLM is employed for two tasks: (1) generating a 52-week seasonal demand curve based on product descriptions; and (2) proposing algorithmic modifications, with the final strategy selected based on a validation score. Regarding (1), why not construct the seasonal curves directly using human-defined priors? Furthermore, why is there no comparison against simple product-category-based rules or seasonal templates? Regarding (2), the final selected strategy (a "capped base-stock" policy) belongs to an existing class of strategies. Why is there no comparison against heuristic search or parameter-tuning methods that do not rely on an LLM?

  2. The organization of the experimental section and the presentation of results lack clarity, making the content difficult to follow. It is recommended that the authors provide an initial, unified overview of the experimental setup. Furthermore, each table should clearly specify the evaluation protocol, sample size, and baseline methods. Finally, the experimental results should be reorganized to better highlight the specific research question addressed by each set of experiments.

Questions for authors

See Weaknesses

1 comment

The authors have not provided a response. Therefore, I will maintain my original score.

Reviewer_GQuzOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

SabreAgent studies lost-sales inventory control where each benchmark instance starts with five historical demand observations and reveals new observations sequentially. It uses a language model at design time to construct product-specific seasonal priors and to help select a capped base-stock policy family for stochastic lead times. During operation, statistical forecasting and operations-research(OR) control choose orders without language-model calls. On 1,320 InventoryBench instances, the method reports an overall normalized reward of 0.6311, compared with 0.5380 for the strongest published baseline, and leads in all six benchmark cells. The ablations show that the frozen OR core accounts for most of the gain, while the two model-authored components provide smaller additional improvements.

Critical strengths
  • On InventoryBench, an independently introduced benchmark with a common evaluator and public baselines, SabreAgent scores 0.6311 versus 0.5380 for the strongest published baseline and leads in all six cells (Table 1).

  • The factorial ablation separates the frozen OR core from the incremental effects of the seasonal and policy-search components (Figure 4).

  • The policy handles lost sales and destroyed orders and makes no language-model calls during operation.

Critical weaknesses
  • The human-designed frozen OR core (forecasting plus inventory control, with the two LLM-authored components disabled) already scores 0.6180 on the batched ablation path, while those components add approximately 0.0138 on that same path (Figure 4). The paper specifies the OR core's rules but does not provide a controlled component-level breakdown explaining its large advantage over public baselines; the published baseline scores are not a same-path OR core ablation.

  • A no-shape ablation does not show whether LLM-generated product shapes outperform directly using the hand-written priors in the elicitation prompt. Capped base-stock is an established family also used by the benchmark's OR baseline (§3.5); an equally tuned, manually selected family would clarify the value of LLM-guided search.

  • The depletion multiplier's functional form was chosen after observing aggregate test-cell mismatches, and repeated reuse of validation instances may introduce adaptive-selection bias (§4.1; Appendix D.4). This does not establish direct access to test trajectories or candidate test scores, but weakens the independence of the final evaluation.

  • InventoryBench assumes no purchase or setup costs for orders and no salvage value for leftover stock (§2.1–2.2). These assumptions suit the paper's cost-based OR design, so benchmark leadership alone does not establish a similar advantage under different operational constraints. This is not a claim that the public benchmark is invalid.

Questions for authors
  • What accounts for the frozen OR core's 0.6180 score? Could you give a controlled, same-evaluator-path breakdown that holds the rest of the system fixed while adding the forecasting mixture, lost-sales pipeline projection, depletion correction, and stochastic-supply modeling? Which changes account for the difference from the public OR baseline?

  • With the forecasting mixture and OR controller fixed, how do the LLM-generated product shapes compare with directly using the hand-written priors already supplied in Appendix D.3? For stochastic supply, how does the selected family compare with an equally tuned, manually chosen capped base-stock family?

  • Can you evaluate the final policy and its key ablations on genuinely untouched instances, given the aggregate test-cell diagnostics used to choose the depletion multiplier's functional form and the repeated validation reuse (§4.1; Appendix D.4)?

  • How sensitive are the method and its baseline comparison to InventoryBench-specific assumptions such as no order purchase costs and no terminal salvage value (§2.1–2.2)? Could you provide results on an independently held-out inventory setting with different cost or operational constraints, or qualify the scope of the generalization claim?

1 comment

As the authors did't engage in the rebuttal phase, I will keep my score.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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