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Under review as a conference paper at ICLR 2027

When Worlds Outlive Scars: How Persistent Environments Carry History Across Agent Resets

Abstract

Resetting an agent does not necessarily reset its learning process. If an earlier policy changed a persistent environment, a fresh policy can inherit a different training distribution even after capability, memory, replay, and parameters have been restored or cleared. We trace the resulting channel from past capability, through a constructed world and fresh post-reset experience, into newly learned parameters and later behavior. Rather than infer this pathway from endpoint correlations, we exchange the intermediate carriers: fresh behavior follows assigned worlds, learned effects follow assigned replay, equalizing full replay removes the parameter contrast, and removing the world after practice preserves it. The inherited contrast is neither intrinsically beneficial nor harmful. Holding the learned snapshots fixed while changing only future task geometry yields positive, negative, and approximately cancelling consequences. An exact model gives a finite regime in which capability composition selects construction, and controlled learned systems realize the pathway without capability labels. The complete lifecycle is established in one designed Fork family; other structures expose explicit failure conditions, so broader carrier validity remains open. Persistent environmental state can therefore act as a hidden history channel even when agent-side state is reset.

Primary area:
reinforcement learning
Keywords:
persistent environments, embodied learning, agent reset, environmental memory, causal interventions, reinforcement learning

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_gR5JOpenReview ↗
Rating
1
Confidence
2
Informativeness
2
Presentation
2
Soundness
1
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Paper summary

This paper introduce an interesting question: whether resetting an agent also removes the effects of its earlier capability changes. The answer can be no: an earlier agent may have changed the world, which then changes what a fresh agent learns. The authors trace this pathway using world swaps, replay swaps, and interventions before and after learning. A small exact model describes when history affects construction. The full pathway is shown in a controlled Fork environment; tests in other environments show where the evidence stops.

Critical strengths

1. The intervention design is the main strength. Swapping the actual worlds and replay buffers, then removing the world after learning, helps pin down where the effect is stored. This gives a concrete way to check what an agent reset does and does not remove.

2. Paper is careful about what its results show. It treats topology skeletons as independent units, reports unsuccessful extensions, and distinguishes a small residual effect from a statistical null. I also found the future-task result helpful: the same learned difference can help on one task and hurt on another.

Critical weaknesses

1. I couldn't reconstruct the central environment from the paper. Sections 4–5 and Appendix D.2 give the network and optimizer, but the four control actions, their transition and reward rules, the collection of the 24 training transitions, and the Fork layouts need more detail. Since the contribution rests on this constructed example, one fully worked instance would make a big difference.

2. The full lifecycle is shown in 12 designed Fork skeletons, but the separate locked audit finds none, even among its 48 Fork variants. These are different experiments, so this isn't a contradiction. Still, I couldn't find a breakdown of which checks fail for that Fork subset. This makes it hard to judge which settings actually support the complete mechanism.

3. Scrubbing the world shows that the learned difference survives removal of its physical cause. It doesn't show how long it survives further learning. The MLP readout uses saved parameters after 400 updates on 24 transitions, without subsequent common experience. Whether the effect persists through further practice or quickly washes out remains unclear.

4. The demand experiment uses two directional tasks and one approximately symmetric task. It shows that the sign can change, but doesn't establish how sensitive the small balanced effect is to less neatly balanced demands. A small asymmetry might make the inherited difference matter again. This limits the practical meaning of cancellation, while leaving the existence result intact.

5. Some figures are hard to read on their own. Figure 2A has no vertical-axis metric label, and its caption doesn't identify the learner. Section 6 points to Figure 3 for the empirical phase scans, but the figure shows the analytic window schematically, with only aggregate coverage counts in the caption. Labeled slices of the actual scan, along with clear metric and learner labels, would make the evidence easier to check.

6. I found it harder than necessary to keep the notation and study versions straight. The symbol d denotes future demand in Eqs. (2)–(3) but healthy cross-method disadvantage in Proposition 1, and 'Fork' covers both the positive lifecycle study and the separate locked audit. Distinct symbols and consistent study labels would make the argument much easier to follow.

Questions for authors

1. Could you provide one complete Fork example, including actions, rewards, transition collection, training targets, and future-task evaluation, with a link to the corresponding artifact?

2. Which checks fail for the 48 Fork variants in the locked audit, and which differences in construction or sampling explain the contrast with the 12 successful Fork skeletons?

3. In the current Fork setup, what happens if both reset agents get the same additional practice before evaluation? Does the effect fade, and if so, how quickly?

4. With the learned snapshots fixed, what happens under small asymmetries in the balanced future task? How much change is needed to move the contrast outside the stated ±0.02 practical region?

Reviewer_DPEXOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
1
Soundness
2
Read review
Paper summary

This paper argues that even when an agent’s body and policy are reset, changes made to the world by an earlier agent can persist and influence subsequent learning. The authors propose a pathway in which a change in capability induces a world modification, the modified world alters a reset agent’s experience, and that experience affects newly learned parameters and performance on future tasks. In a controlled Fork environment, they probe successive stages of this pathway through world swaps, Replay Swaps, replay equalization, and changes to the timing of world scrubbing. They also analyze the cost conditions under which construction is selected and examine where the pathway holds or breaks down in other map structures and Minecraft. Positive evidence for the complete pathway is concentrated in a designed Fork family.

Critical strengths
  1. The paper tests the proposed pathway through direct interventions on its intermediate stages. It examines whether fresh experience follows the assigned world, whether learning outcomes follow the assigned replay, and whether the effect persists after the world modification is removed following learning. These interventions provide stronger evidence than inferring the mechanism from final performance differences alone and help assess the paper’s central claim of a world → experience → parameter pathway.

  2. The paper reports conditions for success alongside failure cases. The authors analyze the range of benefits and costs under which capability-specific construction is selected, and show that the necessary conditions may fail in other map structures. These results help define the mechanism’s scope and support interpreting the claim as a controlled existence result.

Critical weaknesses
  1. The significance and generality of the main result remain limited. Success of the complete pathway is concentrated in a Fork family designed to satisfy the required conditions, while none of the 144 separately generated variants satisfies all the prerequisites for testing the full pathway. The Minecraft experiment reaches only the initial world-modification stage. Moreover, the finding that practice along one direction benefits a future task requiring that direction is largely expected. It is therefore unclear what new insight the study provides beyond establishing that the mechanism can occur in a controlled setting.

  2. The concrete setup of the central experiments is insufficiently conveyed. Sections 4 and 5 make it difficult to understand the maps and tasks being used, how the two capability changes affect actual actions, and how block placements alter routes and experience. The paper also does not show concretely how the geometries of the three future-demand tasks differ. The conceptual schematic and result plots alone make it difficult to assess how the experiments work and how dependent the findings are on their design. A worked example showing capability dependent block placements, post-reset trajectories, and evaluation tasks on the same map would be valuable. The Section 6 end-to-end comparison would also benefit from a clearer account of the two approaches’ inputs and training conditions.

Questions for authors
  1. Could you provide a concrete example of the experiments in Sections 4 and 5? A single example showing the base map and task, how each capability change affects the two primitives, where blocks are placed under each condition, the resulting post-reset routes and experiences, and the geometries of the three future tasks would help readers assess the central experiments.

  2. Why do the designed Fork cases support the complete pathway while none of the 144 separately generated variants meets all its prerequisites? Please clarify how the positive cases were selected and which prerequisites most often prevent the other variants from qualifying.

Reviewer_MA7MOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper investigates how persistent changes to an environment can carry information about an agent's past capability state across agent resets and influence subsequent learning. The authors propose a causal pathway from capability history to persistent world modifications, fresh post-reset experience, newly learned parameters, and future task performance. To investigate this mechanism, the paper introduces several carrier-level interventions, including world swapping, replay swapping, replay equalization, and environmental scrubbing before or after learning. The authors further demonstrate that the same learned parameter differences can have positive, negative, or approximately cancelling effects depending on future task demands. A theoretical analysis characterizes a finite regime in which capability-dependent construction occurs, while experiments examine both successful realizations and structural failure conditions.

Critical strengths

S1. I find the research question interesting and the proposed perspective meaningful. The paper highlights that resetting an agent's parameters and memory does not necessarily eliminate the influence of its past experience, since persistent environmental modifications may continue to shape the data encountered by future agents. I particularly appreciate the intervention-based experimental design. Rather than relying solely on correlations between past capability conditions and subsequent performance, the authors explicitly manipulate intermediate carriers through world swaps, replay swaps, and environmental scrubbing. These interventions provide useful evidence for understanding how historical information propagates through the environment and eventually influences newly learned parameters.

S2. The paper goes beyond demonstrating a positive result by investigating the conditions under which the proposed mechanism can or cannot occur. The theoretical construction window provides an interpretable characterization of capability-dependent environmental modification. I also appreciate the demand-dependent evaluation, which shows that inherited experience is not necessarily beneficial and can lead to different outcomes depending on future tasks. Another positive aspect is the transparent reporting of negative results, including the cross-generator evaluations and unsuccessful extensions to other physical environments. These analyses help clarify the scope of the proposed mechanism and provide potentially useful insights for future research on persistent environments and agent learning.

Critical weaknesses

W1. My main concern is that the complete causal pathway is demonstrated only in one carefully constructed Fork environment family. Although the authors explore several additional environment structures, the broader evaluation provides limited evidence that the same mechanism can emerge in more general settings. In particular, Section 7 reports that none of the 144 variants in the separate cross-generator audit satisfies all the requirements for the complete lifecycle. Furthermore, the Minecraft experiments establish only the upstream persistence and world-intervention mechanisms, without demonstrating the subsequent experience-to-parameter learning process. The tabletop-clutter extension also stops before capability-conditioned evaluation. I appreciate that the authors explicitly acknowledge these limitations. However, the narrow range of successful realizations makes it difficult to assess how broadly applicable or practically significant the proposed mechanism is. Given that persistent environmental effects and distribution shifts are already well-established concepts, I think stronger evidence beyond the specifically designed environment would be important for establishing the broader contribution of this work.

W2. Although the paper aims to understand how persistent environments influence subsequent agent learning, the main downstream learning experiments rely on relatively simple and controlled learning mechanisms. For example, the nonlinear learning experiment uses a small MLP trained on 24 collected transitions with 400 deterministic full-buffer updates. As the authors acknowledge, this is not an online deep RL setting. In addition, the construction process relies on explicit planning and structured state representations, while the future-demand experiments use geometries specifically designed to emphasize different practiced directions. These choices are reasonable for isolating the proposed causal mechanism, but they also limit the conclusions that can be drawn about more realistic learning agents. In particular, it remains unclear whether similar history-dependent effects would persist under online policy learning, noisy or partial observations, and more diverse future task distributions.

Questions for authors

Q1. Could the authors further clarify how the 12 Fork topology skeletons and 22 eligible variants used in the main causal experiments were selected? In particular, how does this selection differ from the separate cross-generator audit, where none of the 144 variants satisfies the complete lifecycle requirements? Understanding these differences would help assess how restrictive the conditions for the proposed mechanism are.

Q2. I would appreciate further clarification regarding the generality of the downstream learning mechanism. The MLP experiment uses one-step reward prediction and deterministic full-buffer optimization rather than online reinforcement learning. Do the authors have evidence that the same experience-to-parameter transfer would persist under online policy learning, or is the current claim intentionally limited to the controlled supervised learning setting?

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