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Under review as a conference paper at ICLR 2027

Direction-Preserving Credit Redistribution for Long-Horizon LLM Agents

Abstract

Long-horizon LLM agents must infer which individual actions deserve credit from sparse trajectory-level outcomes. Existing step-level estimators provide finer-grained supervision, yet the resulting credit is not uniformly reliable: which parts of these signals should the policy trust? We reveal a complementary asymmetry between non-parametric and parametric credit. Non-parametric advantages, derived from realized-return contrasts, provide informative update directions, but their magnitudes remain coupled to sampled continuations and can misallocate credit across actions. Conversely, accurate value or reward estimation is difficult in long-horizon agentic tasks, causing parametric prediction errors to propagate into policy advantages and even reverse update directions; nevertheless, learned value movement retains useful information about relative action contribution. Based on this observation, we introduce Grounded Relative-Value Advantage Weighting (GRAW), a plug-in for non-parametric step-level estimators. GRAW retains the base credit as a grounded allocation prior and uses learned relative value movement only to reweight actions within the same update direction, preserving every base advantage sign and the total absolute credit in each direction. Across three long-horizon agent benchmarks and multiple model scales, GRAW consistently improves strong non-parametric step-level baselines, achieves the best overall performance, reduces variance across seeds, and adds only minimal computational overhead.

Primary area:
reinforcement learning
Keywords:
LLM Agents, Reinforcement Learning, Credit Assignment, Group-Relative Policy Optimization, Long-Horizon Decision Making

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.67 over 3 reviews, above 70% of the others.
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3(+1)
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Paper summary

The paper proposes Grounded Relative-Value Advantage Weighting (GRAW), a plug-in for step-level credit assignment in long-horizon LLM agents. Its motivation is an empirical asymmetry: non-parametric advantages retain informative signs despite noisy magnitudes, while learned value movements provide relative ranking information despite unreliable direct credit estimates. GRAW trains a lightweight value head on detached policy representations using rollout-derived targets, then uses predicted value movements to reweight existing advantages within each trajectory. Positive and negative credits are redistributed separately, preserving every original advantage sign and the total absolute credit in each group. The method is evaluated with GiGPO and HGPO on WebShop, ScienceWorld, and ALFWorld using Qwen2.5 models from 1.5B to 7B. Validation includes Monte Carlo credit diagnostics, ranking agreement with environment-progress proxies, ablations, and computational-cost measurements. The reported results show performance improvements with limited additional computation and no extra rollouts.

Critical strengths
  1. The authors present a diagnostic finding that the signs of credit estimates are more reliable than their magnitudes, which I find reasonably well supported.

  2. The authors conduct extensive evaluations, including multiple-seed experiments and ablation studies. Overall, the conclusions are supported to some extent. I particularly appreciate the method’s control over credit magnitudes, as some studies suggest that these magnitudes can substantially affect performance, with even randomized credit assignment outperforming standard GRPO.

Critical weaknesses

I still recommend rejecting this paper. I believe the authors’ understanding of credit assignment may be somewhat misguided, and the paper’s central insight—that credit magnitudes are unreliable—has already been explored in closely related work. The experimental scope is also relatively narrow and does not adequately establish the method’s general applicability. Please see the Questions for Authors for further details.

Questions for authors

Please address the following questions:

  1. In lines 157–158, you state that the reference advantages in Figure 1 are estimated using 32 continuation rollouts. This number may be insufficient; please consider using more samples, such as 64, to assess the robustness of the findings. Figure 1 is useful and directly illustrates your central idea. However, GiGPO and HGPO are closely related methods from the same family, which limits the breadth and generalizability of the evidence. I accept GiGPO as a representative non-parametric credit assignment method, but analyzing a substantially different approach, such as TreeGRPO, could considerably strengthen the paper.

  2. In Figure 2, the PPO critic’s MAE appears to increase during training, suggesting that its prediction accuracy deteriorates. However, the PPO results in Table 1 do not appear to differ substantially from those of GRPO. Could you explain this relationship? One possible explanation is that success rates are initially low, making many reference values close to zero and consequently yielding a lower MAE early in training.

  3. I am concerned that the paper’s interpretation of credit assignment may be somewhat misguided. Assigning a higher advantage to an action should indicate that it is relatively better than other actions at the same state, rather than merely producing greater absolute progress. For example, under the current policy π\pi, an action at state ss may make only modest progress but still deserve a large advantage if the other available actions perform much worse. This relative comparison is central to methods such as GiGPO. In Figure 3, however, you evaluate the ordering of redistribution multipliers among actions within a trajectory using within-trajectory progress as the reference. I do not find this evaluation sufficiently convincing: credit assignment concerns an action’s advantage relative to alternative actions in group-based methods, or relative to the state-value baseline in PPO-style methods, rather than the amount of progress alone. Could you justify this evaluation criterion and directly assess whether redistribution improves agreement with reference advantages?

  4. Regarding the method itself, the central insight—that credit estimates produced by existing credit assignment algorithms can be unreliable—appears closely related to prior work [1, 2]. I did not find direct comparisons with these methods in the paper. Nevertheless, the observation that advantage signs can be more reliable than their magnitudes provides an additional insight that I find intuitively plausible. Could you clarify the contribution beyond these works and provide appropriate comparisons?

[1] When Denser Credit Is Not Enough: Evidence-Calibrated Policy Optimization for Long-Horizon LLM Agent Training.

[2] StepOPSD: Step-Aware Online Preference Distillation for Agent Reinforcement Learning.

6 comments
AuthorsOpenReview ↗

Response to Q1

Q1. Robustness and Generalizability of Non-parametric Credit Analysis

We thank the reviewer for suggesting a more robust and broader evaluation of non-parametric credit reliability. To address these concerns, we extended the analysis in Fig. 1 in two ways: (1) increasing the number of MC continuations from 32 to 64, and (2) evaluating Tree-GRPO [1], a structurally different non-parametric credit assignment method. We examine both directional reliability and the dependence of empirical credit on sampled outcomes.


(1) Directional Reliability with 64 MC Continuations

We evaluate the sign agreement between non-parametric advantages and MC reference advantages across training checkpoints for GiGPO and Tree-GRPO.

Table A. Sign agreement with MC reference advantages using 64 continuations (95% CIs).

Training StepGiGPOTree-GRPO
250.552 [0.508, 0.592]0.532 [0.476, 0.591]
500.563 [0.527, 0.596]0.610 [0.564, 0.656]
750.648 [0.585, 0.694]0.552 [0.507, 0.600]
1000.667 [0.632, 0.708]0.614 [0.561, 0.674]
1250.770 [0.668, 0.867]0.709 [0.617, 0.791]
1500.826 [0.789, 0.896]0.652 [0.592, 0.722]

GiGPO's sign agreement increases from 0.552 at step 25 to 0.826 at step 150, with the lower bounds of all 95% CIs exceeding 0.5. Tree-GRPO also achieves sign agreement above 0.5 at all six checkpoints, with confidence intervals excluding 0.5 at five of them. Although its sign agreement is generally lower than GiGPO's, these results suggest that Tree-GRPO also provides useful directional information, consistent with the observation in Fig. 1(a).


(2) Dependence of Empirical Credit on Sampled Outcomes

We further quantify the outcome dependence illustrated in Fig. 1(b). We fit linear regressions with the empirical advantage ABA^B as the dependent variable and examine how much additional variance is explained by the realized trajectory outcome after accounting for the MC reference advantage.

Specifically, R2R^2 denotes the coefficient of determination, measuring the proportion of variance in ABA^B explained by a regression model. We define

R2(MC)≔R2(AB∼A^π),R^2(\mathrm{MC}) \coloneqq R^2(A^B\sim\hat A^\pi), R2(MC+Outcome)≔R2(AB∼A^π,Y),R^2(\mathrm{MC+Outcome}) \coloneqq R^2(A^B\sim\hat A^\pi,Y), K≔R2(MC+Outcome)−R2(MC).K \coloneqq R^2(\mathrm{MC+Outcome})-R^2(\mathrm{MC}).

Here, A^π\hat A^\pi is the MC reference advantage, and YY is the binary trajectory outcome (success or failure). R2(MC)R^2(\mathrm{MC}) measures the variance in empirical credit explained by MC reference advantages alone, while R2(MC+Outcome)R^2(\mathrm{MC+Outcome}) measures the variance explained when trajectory outcomes are additionally included. Their difference, KK, quantifies the additional explanatory power of realized outcomes beyond MC reference advantages.

Table B. Outcome dependence of GiGPO and Tree-GRPO credit using 64 MC continuations.

MethodStepR2(MC)R^2(\mathrm{MC})R2(MC+Outcome)R^2(\mathrm{MC+Outcome})KK [95% CI]
GiGPO250.0910.7130.622 [0.516, 0.698]
500.0940.5290.435 [0.347, 0.517]
750.1520.4210.269 [0.185, 0.360]
1000.1320.5070.375 [0.294, 0.455]
1250.2860.4550.169 [0.060, 0.299]
1500.0830.3480.265 [0.082, 0.462]
Tree-GRPO250.0540.2800.226 [0.066, 0.443]
500.1700.8030.632 [0.561, 0.719]
750.1570.6780.521 [0.438, 0.619]
1000.1620.7220.560 [0.473, 0.665]
1250.1850.4780.293 [0.131, 0.490]
1500.1740.5990.425 [0.293, 0.587]

For GiGPO, MC reference advantages alone explain relatively little variation in empirical credit (R2(MC)=0.083R^2(\mathrm{MC})=0.083–0.2860.286), while adding trajectory outcomes increases explained variance by K=0.169K=0.169–0.6220.622. Some outcome dependence is expected because GiGPO explicitly incorporates trajectory-level credit. Nevertheless, realized outcomes explain substantial additional variation even after accounting for MC reference advantages, consistent with Fig. 1(b).

Tree-GRPO exhibits a similar pattern. MC reference advantages alone explain only 0.054–0.185 of the variation in empirical credit, while trajectory outcomes provide an additional explained variance of K=0.226K=0.226–0.6320.632. Thus, the dependence on sampled outcomes persists in a structurally different non-parametric estimator, suggesting that this phenomenon is not specific to GiGPO's credit construction.

These results support the two observations in Fig. 1: non-parametric advantages provide useful directional information, but their estimated credit values remain associated with the outcomes of individual sampled trajectories. Importantly, these patterns are observed with 64 MC continuations and extend beyond the GiGPO/HGPO family to Tree-GRPO. We will include these additional analyses in the revised manuscript.

[1] Ji, Yuxiang, et al. "Tree search for llm agent reinforcement learning." International Conference on Learning Representations. 2026.

AuthorsOpenReview ↗

Response to Q2

Q2. Critic Value Error and PPO Performance

As noted in Sec. 3.2, increasing MAE partly reflects a broader distribution of MC reference values as the policy improves. We provide further analysis to clarify this trend and its relationship to PPO's performance.


(1) Interpreting the Increase in Critic MAE

We analyzed the PPO critic on WebShop (seed 0) across training checkpoints.

Table A. PPO critic evaluation against MC reference state values.

StepSuccess RateMC Value (Mean ± Std.)Critic MAERelative SkillPearson Corr.
2510%0.10 ± 0.160.101−0.020.23
5031%0.23 ± 0.280.193+0.150.53
10060%0.42 ± 0.330.247+0.170.69
15067%0.52 ± 0.370.192+0.390.77

Relative skill measures the critic's MAE improvement over a baseline that predicts the same constant value for every state:

Skill=1−MAE(critic)MAE(best constant).\mathrm{Skill}=1-\frac{\mathrm{MAE}(\mathrm{critic})}{\mathrm{MAE}(\mathrm{best\ constant})}.

The best constant is the median MC reference value, which minimizes MAE among constant predictions. Thus, a skill of zero indicates performance equal to this baseline, while positive values indicate better predictions. Pearson correlation measures the correlation between critic predictions and MC reference state values.

At step 25, the success rate is only 10%, and MC reference values are concentrated near zero (0.10 ± 0.16). Predicting zero for every state yields an MAE of 0.100, nearly identical to the critic's MAE of 0.101. As training progresses, the MC value mean increases from 0.10 to 0.52, while its standard deviation grows from 0.16 to 0.37. Thus, reference values become larger and more dispersed, contributing to higher absolute prediction errors.

Despite the initial increase in MAE, the critic's relative skill improves from −0.02 to +0.39, indicating 39% lower MAE than the best constant baseline at step 150. Its Pearson correlation also increases from 0.23 to 0.77. These results suggest that the higher MAE reflects changes in the reference-value distribution rather than deteriorating state-value prediction. Nevertheless, despite improvements in relative skill and correlation, the critic still exhibits substantial absolute prediction errors, and the resulting PPO advantages frequently disagree in sign with MC reference advantages (Fig. 2).


(2) Explaining the Performance Similarity Between PPO and GRPO

Despite substantial critic prediction errors and frequent advantage sign disagreements, PPO performs similarly to GRPO. To understand this, we examine how PPO advantages are computed and how they depend on realized trajectory outcomes.

In our PPO configuration, advantages are computed using generalized advantage estimation (GAE), which aggregates temporal-difference (TD) residuals:

\qquad A_t^{\mathrm{PPO}} = \sum_{\ell=0}^{T-t}(\gamma\lambda)^\ell\delta_{t+\ell}.$$ Here, $V_\phi$ is the learned critic, and $\lambda$ controls the contribution of subsequent residuals. In sparse-reward environments, where rewards are given only at the terminal step $T$, the terminal reward $R$ contributes to preceding advantages through $(\gamma\lambda)^{T-t}R$. Thus, although GAE incorporates state-dependent value predictions, its advantage estimates remain strongly influenced by the realized trajectory outcome. **Consequently, critic prediction errors do not necessarily lead to proportional performance degradation, as realized trajectory outcomes still provide a substantial learning signal.** To verify this dependence, we compared two predictors of PPO advantage signs: an outcome-based predictor that assigns positive signs to actions in successful trajectories and negative signs to those in failed trajectories, and the MC reference advantage signs. Both were evaluated on the same actions with nonzero MC reference advantages. Across six checkpoints, the outcome-based predictor agrees with PPO advantage signs in 86.6–100% of cases, compared with only 52.8–60.1% for MC reference signs. The difference is 33.8–41.1 percentage points, with trajectory-bootstrap 95% CIs excluding zero at every checkpoint. These results show that PPO's credit directions are much more closely associated with realized trajectory outcomes than with the relative contributions of individual actions. **These findings help explain why PPO can achieve performance comparable to GRPO despite imperfect critic predictions.** PPO can still learn from trajectory-level outcomes even when its critic is inaccurate. However, as shown in Fig. 2(b), this does not necessarily provide reliable action-level credit, since learned advantages can assign incorrect update directions. Meanwhile, Fig. 2(c) shows that learned value movements retain useful relative ranking information. This motivates GRAW to preserve the update directions of non-parametric advantages while using learned value movements to refine their relative allocation.
AuthorsOpenReview ↗

Response to Q3

Q3. Justification and Validation of Credit Redistribution

We thank the reviewer for this point. We agree that policy advantage measures an action's value relative to alternatives at the same state, rather than its absolute environment progress. We clarify how GRAW relates to this definition and why Fig. 3 provides a meaningful evaluation of credit redistribution.


(1) Policy Advantage and Empirical Credit Estimation

In RL, the action-value function Qπ(st,at)Q^\pi(s_t,a_t) measures the expected return after taking action ata_t at state sts_t, while the state-value function Vπ(st)V^\pi(s_t) averages returns over actions sampled from the same policy. The true advantage is defined as

Aπ(st,at)=Qπ(st,at)−Vπ(st).A^\pi(s_t,a_t)=Q^\pi(s_t,a_t)-V^\pi(s_t).

GiGPO and HGPO approximate this relative comparison by contrasting a single realized return for each action against empirical baselines constructed from matching-state visits. In contrast, the true action value Qπ(st,at)=E[Gt∣st,at]Q^\pi(s_t,a_t)=\mathbb{E}[G_t\mid s_t,a_t] averages over possible future continuations. Although these empirical contrasts can provide informative update directions, as shown in Fig. 1(a), their magnitudes remain influenced by downstream decisions in the sampled continuation. Consequently, non-parametric advantages can provide useful directional guidance while misallocating credit magnitudes across actions.

To mitigate this limitation, GRAW separates update direction from credit magnitude. The base non-parametric advantage determines whether an action is reinforced or suppressed, while learned value movements determine how much credit is assigned to each action. GRAW redistributes credit within each trajectory and update-direction group, preserving both the original advantage signs and the total credit magnitude of each group.

Under deterministic transitions and zero intermediate rewards, the true advantage at an intermediate step satisfies

Aπ(st,at)=γVπ(st+1)−Vπ(st).A^\pi(s_t,a_t)=\gamma V^\pi(s_{t+1})-V^\pi(s_t).

This motivates GRAW's learned value movement mt=γVϕ(st+1)−Vϕ(st)m_t=\gamma V_\phi(s_{t+1})-V_\phi(s_t), which serves as a relative reweighting signal rather than a direct estimate of advantage.


(2) Justification of the Progress-Based Evaluation in Fig. 3

Although environment progress is not equivalent to policy advantage, Fig. 3 evaluates a specific aspect of GRAW's redistribution mechanism. GiGPO and HGPO already incorporate relative comparisons against sampled alternatives at matching states when constructing their base advantages. GRAW preserves the resulting update directions and only redistributes credit magnitudes among actions sharing the same direction.

Accordingly, Fig. 3 examines whether GRAW assigns larger multipliers to actions associated with greater environment progress in positive-credit groups, or larger decreases in progress in negative-credit groups. This evaluation focuses on how learned values guide the relative allocation of existing credit, rather than determining whether an action is better or worse than alternatives at the same state.

We acknowledge that progress-based evaluation does not directly establish agreement with true policy advantages, as actions with similar environment progress may have different advantages depending on the alternatives available at their respective states. We therefore complement Fig. 3 with a direct comparison against Monte Carlo reference advantages, as presented below.


(3) Direct Validation Against Monte Carlo Reference Advantages

To directly address the reviewer's concern, we evaluate whether GRAW's redistribution improves agreement with MC reference advantages rather than merely environment progress. We conducted this evaluation on GiGPO+GRAW with 64 MC continuations at six checkpoints. Pairwise ranking accuracy and Spearman correlation are measured within each trajectory and base advantage direction group, matching the scope of GRAW's credit redistribution.

The final GRAW advantages achieve better ranking agreement with MC references than the base advantages at all six checkpoints. Average pairwise ranking accuracy increases from 0.594 to 0.624, while within-trajectory Spearman correlation increases from 0.161 to 0.287.

These improvements arise from the complementary roles of the two signals. The base advantages provide more reliable update directions than the learned head movements, with average sign agreement of 0.678 vs. 0.504. In contrast, the learned head provides better relative ranking information, achieving pairwise accuracy of 0.634 vs. 0.594 for the base advantages. GRAW preserves base advantage signs and uses learned value movements to redistribute credit magnitudes.

These results show that GRAW achieves better ranking agreement with MC reference advantages, complementing the progress-based analysis in Fig. 3. Detailed results, including trajectory-bootstrap confidence intervals, are provided in our response to Reviewer qcG2 (W1).

Reviewer_qcG2OpenReview ↗
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3
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2
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2
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Paper summary

This paper proposes GRAW, a plug-in framework for improving step-level credit assignment in long-horizon LLM agents. The authors identify a complementary asymmetry between non-parametric and parametric credit estimators: non-parametric advantages provide informative update directions but suffer from inaccurate credit magnitudes, while learned value estimates offer useful relative action rankings despite unreliable direct credit estimation. GRAW combines these signals by using learned relative value movements to reweight non-parametric advantages while preserving their signs and total absolute credit within each direction. Experiments on WebShop, SciWorld, and ALFWorld demonstrate consistent improvements over GiGPO and HGPO across multiple model scales, with reduced training variance and minimal computational overhead.

Critical strengths
  • Clear motivation and empirical analysis. The method is well motivated, supported by detailed empirical analyses that provide evidence for the complementary strengths of non-parametric advantage directions and parametric relative-value rankings.

  • Consistent empirical improvements. GRAW consistently improves two strong step-level RL baselines (GiGPO and HGPO) across three benchmarks and multiple model scales. The ablation studies further support the effectiveness of the proposed design choices.

  • Computational efficiency and practicality. By reusing policy representations through a lightweight value head, GRAW avoids the overhead of a separate critic backbone. Its plug-in design makes it practical to integrate into existing step-level RL algorithms.

Critical weaknesses
  • Insufficient validation of the complementary reliability assumption. The paper separately examines the directional reliability of non-parametric advantages and the ranking quality of parametric value movements, but does not directly compare both signals under a unified evaluation protocol. Moreover, the parametric analysis in Section 3 uses a PPO critic rather than the lightweight value head employed by GRAW.

  • Limited comparisons with alternative credit-reweighting strategies. Although the paper includes an additive integration baseline, comparisons with other multiplicative reweighting strategies, such as random reweighting, value-level weighting, and reweighting without direction-wise credit conservation, are missing. These comparisons would help clarify which components are responsible for the observed improvements.

  • Moderate reliability of learned action rankings. The pairwise ranking accuracy in Figure 3 ranges from approximately 0.57 to 0.70. While consistently above chance, these results indicate that the learned rankings remain relatively noisy.

Questions for authors

See Weaknesses.

5 comments
AuthorsOpenReview ↗

Response to W1

W1. Unified Evaluation of Non-parametric and Learned Credit Signals

We thank the reviewer for this important suggestion. We agree that a unified evaluation would provide stronger evidence for the complementary reliability of non-parametric advantages and learned value movements. Moreover, the PPO critic analyzed in Sec. 3 differs from the lightweight value head used by GRAW.

To address these concerns, we conducted an additional analysis on GiGPO+GRAW (WebShop) using Monte Carlo (MC) reference advantages estimated from 64 continuation rollouts. We evaluate the base non-parametric advantages, the actual GRAW value-head movements, and the final redistributed advantages on the same on-policy trajectories against the same MC references.


(1) Directional Reliability of Base Advantages and Learned Value Movements

We first compare the sign agreement of the base advantage and the GRAW head movement mtm_t against MC reference advantages. The evaluation includes steps with nonzero base credit.

Table A. Sign agreement with MC reference advantages (trajectory-bootstrap 95% CIs).

Training StepBase AdvantageGRAW Head Movement
250.600 [0.569, 0.633]0.491 [0.453, 0.530]
500.610 [0.577, 0.645]0.515 [0.474, 0.555]
750.641 [0.609, 0.676]0.443 [0.402, 0.483]
1000.629 [0.591, 0.669]0.532 [0.494, 0.571]
1250.730 [0.684, 0.776]0.559 [0.493, 0.628]
1500.858 [0.818, 0.898]0.486 [0.435, 0.535]

The base advantages consistently show higher sign agreement than the learned movements across all checkpoints, averaging 0.678 versus 0.504. Notably, base sign agreement increases to 0.858 at step 150, while the head remains close to chance. This supports our observation that non-parametric advantages provide more reliable update directions, whereas learned value movements are less suitable for directly determining policy credit.


(2) Relative Ranking Reliability and Credit Redistribution Quality

We next evaluate whether these signals capture relative action quality within each trajectory and base advantage direction group. We compare the base advantage, GRAW head movement, and final GRAW advantage against the same MC reference advantages using pairwise ranking accuracy and within-trajectory Spearman correlation.

Table B. Pairwise ranking accuracy against MC reference advantages (trajectory-bootstrap 95% CIs).

StepBaseHead MovementGRAW Advantage
250.565 [0.542, 0.590]0.613 [0.579, 0.645]0.574 [0.543, 0.603]
500.585 [0.563, 0.608]0.636 [0.598, 0.673]0.602 [0.566, 0.636]
750.605 [0.573, 0.639]0.602 [0.566, 0.633]0.617 [0.582, 0.654]
1000.589 [0.559, 0.623]0.628 [0.593, 0.660]0.602 [0.572, 0.635]
1250.648 [0.601, 0.699]0.632 [0.571, 0.693]0.653 [0.594, 0.715]
1500.569 [0.526, 0.611]0.690 [0.642, 0.732]0.696 [0.645, 0.743]

Table C. Within-trajectory Spearman correlation with MC reference advantages (trajectory-bootstrap 95% CIs).

StepBaseHead MovementGRAW Advantage
250.188 [0.096, 0.285]0.203 [0.101, 0.305]0.275 [0.184, 0.370]
500.180 [0.103, 0.254]0.136 [0.043, 0.212]0.306 [0.237, 0.377]
750.125 [0.038, 0.206]0.217 [0.106, 0.268]0.284 [0.204, 0.363]
1000.118 [0.031, 0.202]0.157 [0.036, 0.254]0.268 [0.189, 0.351]
1250.169 [0.040, 0.288]0.225 [0.107, 0.354]0.398 [0.285, 0.518]
1500.185 [0.040, 0.326]0.120 [0.018, 0.154]0.191 [0.039, 0.333]

The learned head movements provide useful relative ranking information despite their unreliable update directions. Averaged across checkpoints, the head achieves a pairwise accuracy of 0.634, compared with 0.594 for the base advantages.

More importantly, the final GRAW advantages achieve higher ranking accuracy and Spearman correlation than the base advantages at all six checkpoints. Average pairwise accuracy increases from 0.594 to 0.624, while Spearman correlation increases from 0.161 to 0.287. These improvements indicate that combining learned relative movements with grounded non-parametric credit produces rankings that better agree with MC reference advantages.

The results also clarify why GRAW does not directly replace the base advantages with learned movements. Although the head provides useful relative information, its directional predictions remain unreliable. GRAW instead preserves the base advantage signs and uses the head only to refine credit allocation within each direction.

AuthorsOpenReview ↗

Response to W2

W2. Comparison with Alternative Credit Reweighting Strategies

We thank the reviewer for suggesting additional comparisons. To examine the contribution of learned relative value movements, we conducted additional experiments on GiGPO + WebShop using three random seeds, comparing GRAW with two alternative reweighting strategies.


(1) Alternative Reweighting Strategies

  • Random reweighting: Randomly permute mtm_t within each trajectory and update-direction group, preserving the distribution of learned movements, advantage signs, and directional credit budgets while removing action-specific ranking information.
  • Value-level weighting: Replace the relative movement mt=γVϕ(st+1)−Vϕ(st)m_t=\gamma V_\phi(s_{t+1})-V_\phi(s_t) with the next-state value Vϕ(st+1)V_\phi(s_{t+1}), while keeping the remaining redistribution procedure unchanged.

(2) Results and Analysis

Table A. WebShop success rates (%) across training checkpoints (mean over three seeds).

StepGRAWRandomValue-level
108.68.37.6
2014.613.516.7
3019.519.322.1
4030.523.730.7
5031.839.832.8
6044.833.939.1
7053.149.052.1
8056.250.555.2
9052.355.549.7
10061.551.056.5
11064.154.758.6
12065.962.064.8
13063.557.856.5
14066.760.258.6
15072.768.868.5
Checkpoint Avg.47.0543.2044.63

Random reweighting retains reasonable performance despite removing learned ranking information. At step 150, it achieves 68.8% success, compared with 72.7% for GRAW. Since random reweighting still preserves advantage signs and directional credit budgets, the policy can continue learning without relying on accurate head rankings. Nevertheless, GRAW outperforms random reweighting at 13 of 15 checkpoints, with an average gain of 3.85 points. This suggests that learned action-specific movements provide additional benefits beyond the structural constraints of redistribution.

Value-level weighting is less effective at emphasizing task-critical actions. Although its checkpoint-average performance is slightly higher than random reweighting, it performs worse at the final three checkpoints. In the inspected training rollouts, next-state values tended to increase as trajectories progressed. Consequently, value-level weighting assigned smaller multipliers to early actions, such as searching and selecting products, when their base advantages were positive. Conversely, when their base advantages were negative, these early actions received larger penalties because their next-state values were relatively low. This can misallocate credit by under-reinforcing important early decisions in successful trajectories and over-penalizing them in failed ones, even when the decisive error occurs later. We also observed more failures involving incorrect product purchases in the value-level runs. These observations suggest that relative value movements provide a more appropriate signal for distinguishing individual action contributions than next-state value levels alone.

GRAW achieves higher final performance than both alternatives, supporting the use of action-specific relative value movements rather than random assignments or absolute next-state values.

We also conducted component-wise ablations of sign preservation, budget preservation, exponential weighting, and direction awareness (see our response to Reviewer eo34, Q3). These ablations help clarify the roles of individual redistribution components and the structural constraints imposed by GRAW. We will include these comparisons in the revised manuscript.

AuthorsOpenReview ↗

Response to W3

W3. Utility of Imperfect Relative Action Rankings

We agree that the learned rankings are not perfectly accurate. Nevertheless, GRAW exploits the useful relative information retained in these noisy signals by redistributing existing non-parametric credit only within the same trajectory and update direction. By preserving advantage signs and directional credit budgets, GRAW limits the influence of ranking errors.

As shown in Fig. 3, pairwise ranking accuracy exceeds chance in 35 of 36 evaluated settings. Although environment-derived progress is an imperfect proxy for action contribution, our additional MC-based analysis in W1 further supports the usefulness of learned relative rankings. Specifically, the head achieves an average pairwise ranking accuracy of 0.634, compared with 0.594 for the base advantages.

Our additional experiments in W2 further demonstrate the practical benefit of learned rankings. Random reweighting preserves the same sign and budget constraints while removing action-specific ranking information. Although this variant maintains reasonable performance, GRAW outperforms it at 13 of 15 checkpoints, achieving 72.7% vs. 68.8% success at the final checkpoint. This suggests that the learned rankings contribute to performance improvements beyond the redistribution constraints alone.

These results indicate that, despite their imperfect accuracy, learned relative rankings provide useful information for refining credit allocation. GRAW leverages this information while retaining the update directions and credit budgets of the base estimator.

We sincerely appreciate your thoughtful feedback, which has helped us clarify our approach. We would welcome any further questions or suggestions and would be happy to provide additional clarification.

Reviewer_eo34OpenReview ↗
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Paper summary

This paper investigates the step-level credit assignment problem in long-horizon reinforcement learning for LLM Agents: non-parametric advantages are directionally reliable but imperfect in magnitude allocation, while using learned values directly as credit is unreliable yet retains relative ordering information. The core method, GRAW, reuses detached policy hidden states with a lightweight value head and performs intra-trajectory, same-direction positive multiplier redistribution of non-parametric advantages according to relative value shifts, preserving the advantage sign and the total absolute credit in each direction. The contribution lies in revealing the complementary asymmetry between the two types of signals and proposing a plug-in, direction-preserving redistribution framework. Experiments on WebShop, SciWorld, and ALFWorld demonstrate its consistent improvement over GiGPO/HGPO, effective across models from 1.5B to 7B parameters.

Critical strengths
  1. The paper systematically reveals through Figures 1 and 2 that the non-parametric advantage direction is reliable, though its magnitude is influenced by sampling continuation; while the absolute learning value is inaccurate, the relative ordering within trajectories is preserved. This observation provides a basis for "redistribution using only the learning signal," avoiding the direct use of the critic as credit. The problem is accurately positioned and offers reference value to the community.
  2. GRAW uses positive multipliers to preserve the sign of each advantage, normalizing separately along positive and negative directions to maintain total absolute credit; zero credit is not created, and redistribution is done only within groups of the same trajectory and same direction. It reuses the policy's hidden state with a lightweight head, requiring no additional rollouts or backbone forward passes, making it easy to integrate into GiGPO/HGPO and practical for engineering purposes.
Critical weaknesses
  1. The research problem of the paper is important, and the observations are valuable. However, the main results on 1.5B HGPO are only 1.44, some metrics are merely 0.00/0.75, and there are only three seeds. There are no paired tests and no sensitivity experiments for (beta), head learning rate, etc., making it difficult to rule out seed noise and tuning gains. The statistical evidence is insufficient to support strong conclusions in a top conference.

  2. The method's plugin has low overhead, and the design to preserve identity and budget is safe. However, the lightweight detached head has limited expressiveness, and continuous updates to the backbone lead to a non-stationary input distribution, making it unclear whether the head can keep up with retraining in each round. The paper does not provide head loss curves, representation drift metrics, frozen controls, or error propagation bounds, making it impossible to ensure that value head reflects the current policy, and the robustness of the core signal is questionable.

Questions for authors
  1. The paper conducted extensive experiments on many benchmarks, but the improvements on the 1.5B model are only 1–2 points or even 0.00, and it only uses 3 seeds, with no paired tests or confidence intervals; this directly determines whether the assertion that 'GRAW is truly superior to the base model' can hold.

  2. The model's value head is lightweight, but this brings limitations in expressiveness, and the backbone is continuously changing; the paper does not provide analyses on head error, representation drift, frozen comparisons, or lag effects. If it cannot keep up with the current policy, reallocation lacks reliable justification.

  3. The design of (alpha_t) is indeed ingenious, composed of sign preservation, budget preservation, exponential bias, and direction awareness, but there are no ablation studies of alternative forms, no error propagation bounds, and no worst-case analyses; hence, it is impossible to determine whether this is a necessary design or merely an arbitrary heuristic.

5 comments
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Response to W1 & Q1

W1 & Q1. Statistical Reliability and Consistency of Performance Gains

We thank the reviewer for raising concerns about the statistical reliability of our improvements. To address potential seed noise, we conducted additional paired analyses using the same random seeds and evaluation checkpoints for each baseline and GRAW.


(1) Seed-Level Paired Comparison

For each seed, we averaged performance across evaluation checkpoints (steps 5–150) and computed the paired difference between GRAW and its corresponding baseline. We then performed two-sided paired t-tests on the three seed-level differences, reporting 95% confidence intervals.

Table A. Seed-level paired improvements averaged across all six evaluation metrics.

MethodSeed 0Seed 1Seed 2Mean Δ95% CIp-value
GiGPO + GRAW+1.90+6.00+2.31+3.40[−2.21, 9.01]0.121
HGPO + GRAW+1.31+1.23+3.29+1.94[−0.96, 4.85]0.102

Both methods show positive average improvements across all three seeds. GiGPO+GRAW achieves an average gain of +3.40 points, while HGPO+GRAW improves by +1.94 points. Although the paired tests do not reach statistical significance with only three seeds, GRAW consistently improves the training-averaged performance across all three seeds for both GiGPO and HGPO.


(2) Checkpoint-Level Consistency

To examine whether these gains depend on particular checkpoints, we further compared GRAW and its corresponding baseline at every evaluation checkpoint from steps 5 to 150. This yields 90 paired observations per benchmark (30 checkpoints × 3 seeds).

Table B. Performance improvements across training checkpoints.

BenchmarkGiGPO Mean ΔImproved PairsHGPO Mean ΔImproved Pairs
WebShop+4.4069/90+3.5965/90
SciWorld+4.3363/90+2.1359/90
ALFWorld+1.4951/90+0.1146/90
Overall+3.4077/90+1.9463/90

Each benchmark reports the average of its two evaluation metrics. Overall averages all six metrics.

GRAW improves performance across most evaluation checkpoints, particularly on WebShop and SciWorld. For GiGPO, the overall performance improves at 77 of 90 seed-checkpoint pairs, while HGPO shows improvements at 63 of 90 pairs. The gains on ALFWorld are less consistent, especially for HGPO. These results indicate that the overall improvements are not restricted to isolated checkpoints but persist across substantial portions of training, consistent with the training dynamics in Fig. 5. Since checkpoints within each training run are correlated, statistical tests are conducted at the seed level rather than treating all 90 checkpoints as independent samples.

To further assess the robustness of GRAW, we are currently conducting sensitivity analyses of the redistribution temperature β\beta and value-head learning rate. We will share the results in a follow-up comment once the experiments are completed.

AuthorsOpenReview ↗

Response to W2 & Q2

W2 & Q2. Stability of Learned Relative-Value Signals under Policy Updates

We thank the reviewer for raising concerns about the reliability of the lightweight value head under continuous policy updates. GRAW does not require accurate absolute value predictions, as it relies on relative value movements. We further examine whether the head remains informative as the policy evolves.


(1) Robustness to Value Calibration Drift

GRAW computes redistribution weights from normalized relative movements zt=sign⁡(AtB)mt/σmz_t=\operatorname{sign}(A_t^B)m_t/\sigma_m, rather than absolute values. This formulation has two invariance properties:

  • Additive-offset invariance: A global shift V′(s)=V(s)+cV'(s)=V(s)+c adds the same term (γ−1)c(\gamma-1)c to all movement scores, which cancels in the within-group normalization.
  • Positive-scale invariance: A global rescaling, V′(s)=aV(s)V'(s)=aV(s), a>0a>0, is canceled by standard-deviation normalization when the numerical stability threshold is not activated.

These invariances reduce GRAW's dependence on precisely calibrated absolute values.


(2) Reliability of the Value Head throughout Training

As described in Algorithm 1, GRAW computes αt\alpha_t using pre-update head predictions on newly collected on-policy rollouts. Since the head has not yet been updated on the current batch, these predictions allow us to assess whether it maintains useful relative information as the policy backbone evolves.

To evaluate this, we measure the within-trajectory Spearman correlation between predicted value movements and movements derived from the outcome-based targets in Eq. 11.

Table A. Spearman correlation between predicted and target value movements (mean over 3 seeds).

Method / BenchmarkSteps 10–50Steps 60–100Steps 110–150
GiGPO+GRAW / WebShop0.180.210.31
GiGPO+GRAW / SciWorld0.150.240.27
GiGPO+GRAW / ALFWorld0.100.160.19
HGPO+GRAW / WebShop0.120.190.28
HGPO+GRAW / SciWorld0.170.200.28
HGPO+GRAW / ALFWorld0.120.180.19

Although modest, the correlations remain positive and increase throughout training, suggesting that the head retains useful relative information despite backbone updates. Consistently, Fig. 3 shows above-chance ranking accuracy in 35 of 36 settings.

We further examine whether this relative information is useful for credit redistribution. In an additional MC-based evaluation using the actual GRAW head (Reviewer qcG2, W1), learned movements achieve a pairwise ranking accuracy of 0.634, compared with 0.594 for the base advantages. The final redistributed advantages also improve ranking agreement with MC references from 0.594 to 0.624. Furthermore, randomly permuting the learned movements while preserving the same sign and budget constraints reduces final WebShop success from 72.7% to 68.8% (Reviewer qcG2, W2).


(3) Within-Iteration Ranking Stability

Although αt\alpha_t is computed before each policy update, the backbone and head continue to change during minibatch optimization. To examine this lag, we compare the predictions used for redistribution with those obtained on the same inputs after the final minibatch update.

Table B. Within-iteration prediction stability (WebShop, seed 0).

Method / MetricSteps 1–50Steps 51–100Steps 101–150
GiGPO+GRAW / Correlation0.830.950.97
GiGPO+GRAW / Pairwise order reversals15%8%5%
HGPO+GRAW / Correlation0.870.950.96
HGPO+GRAW / Pairwise order reversals11%8%6%

After the first 50 steps, correlations remain around 0.95 or higher, with only 5–8% of action pairs reversing their ordering. This suggests that rankings remain largely stable during policy updates.


(4) Expressiveness–Efficiency Trade-off

The lightweight head is designed to provide relative action information without the cost of a separate critic backbone. As shown in Figs. 4 and 9, replacing it with a full-backbone critic improves average performance by only +0.9/+0.2 points for GiGPO/HGPO. We further measured the computational overhead using a separate Qwen2.5-1.5B critic. Critic forward and update operations alone add computation equivalent to 34–41% of GRAW's training-step time on WebShop and 60–63% on ALFWorld. GPU model computation increases by 1.9–3.2×, with an additional 8–9 GB of peak memory per GPU.

In contrast, GRAW uses a 0.6M-parameter head that reuses policy hidden states without additional backbone forward passes. Its redistribution computation takes only 0.78–0.83 seconds per step on ALFWorld (Fig. 6), less than 1% of the training-step time. The small performance difference relative to the full critic suggests that shared policy representations already contain useful information for relative action discrimination, making the lightweight head a reasonable efficiency–performance trade-off.

These results suggest that the lightweight head provides useful relative ranking signals despite ongoing backbone updates.

AuthorsOpenReview ↗

Response to Q3

Q3. Design Principles and Robustness of Credit Redistribution

We thank the reviewer. We justify αt\alpha_t with a KL formulation, ablations, and robustness bounds.

Principled formulation. GRAW's exponential redistribution can be derived as the closed-form solution to a KL-regularized optimization problem: max⁡q∈Δ(Gd)∑tqtzt−βDKL(q∥p).\max_{q \in \Delta(G^d)} \sum_t q_t z_t - \beta D_{\mathrm{KL}}(q\|p). Here pt=∣AtB∣/Mdp_t=|A_t^B|/M^d is normalized base credit. The solution qt∝ptexp⁡(zt/β)q_t \propto p_t\exp(z_t/\beta) recovers Eq. 16, justifying exponential weighting and budget preservation.


(1) Component-Wise Ablations

We conducted additional ablations on GiGPO + WebShop, modifying one component at a time while keeping all other settings identical:

  • w/o sign preservation: We replace multiplicative reweighting with zero-sum additive credit transfers, matching GRAW's groupwise L1 transfer magnitude and transfer directions. This allows small-magnitude advantages to change sign.
  • w/o budget preservation: We remove the direction-wise normalization and directly apply αt=exp⁡(zt/β)\alpha_t=\exp(z_t/\beta), allowing credit mass to change.
  • w/o exponential tilt: We replace exponential weighting with a linear tilt based on chi-squared regularization, using the same temperature and normalization.
  • w/o direction awareness: We remove the advantage-sign factor and use zt=mt/σmz_t=m_t/\sigma_m for both positive and negative groups, reversing the intended score ordering for negatively credited actions.

Table A. Component-wise ablation results on GiGPO + WebShop (three seeds).

MethodScoreSuccessΔ ScoreΔ Success
GRAW90.16 ± 0.2875.52 ± 1.63——
w/o sign preservation88.74 ± 1.1776.82 ± 1.97−1.42+1.30
w/o budget preservation89.88 ± 1.6976.30 ± 1.63−0.28+0.78
w/o exponential tilt86.22 ± 3.1873.96 ± 2.74−3.94−1.56
w/o direction awareness84.67 ± 2.6271.09 ± 1.35−5.49−4.43

Direction awareness has the largest impact. Removing it decreases score by 5.49 points and success by 4.43 points, consistently across all three seeds. This confirms the importance of interpreting value movements according to the base advantage direction.

Exponential weighting also contributes to performance. Replacing it with linear weighting reduces score by 3.94 points across all seeds, despite nearly identical redistribution strength (0.99–1.00×). This suggests that the nonlinear allocation provides benefits beyond simply adjusting credit magnitude.

Sign and budget preservation provide structural safeguards rather than consistent performance gains. Removing either leads to small and mixed performance changes. Under the default setting, removing sign preservation reverses only 0.1–0.3% of action signs, which helps explain the limited performance difference. In contrast, the additive integration baseline in Sec. 5.5 reverses approximately 10% of signs and substantially degrades performance. Similarly, removing budget normalization changes groupwise credit mass by up to 22%, although final performance remains comparable. These results suggest that sign and budget preservation are not the primary drivers of performance gains in the tested setting, but provide explicit guarantees that learned predictions cannot reverse base advantage signs or change directional credit budgets.


(2) Worst-Case Guarantees and Error Propagation

For arbitrary head predictions, GRAW exactly preserves the sign and directional credit budget:

\qquad \sum_{t\in G^d}|A_t^{\mathrm{GRAW}}|=M^d.$$ Let $\Delta_z$ denote the maximum within-group range of normalized scores. The redistribution is bounded by $$e^{-\Delta_z/\beta}\leq\alpha_t\leq e^{\Delta_z/\beta}.$$ This bound limits how much each advantage can be amplified or reduced, with larger $\beta$ keeping the redistributed credit closer to the base allocation. Furthermore, consider a perturbation in value-head predictions, $e_t=\hat V(s_t)-V(s_t)=c_\tau+\eta_t$, where $c_\tau$ is a trajectory-wise constant bias and $\eta_t$ is the state-dependent residual error. With fixed normalization $\sigma_m$, the constant bias cancels within each group, and the residual error, bounded by $|\eta_t|\leq\epsilon$, satisfies $$\left|\log\frac{\hat{\alpha}_t}{\alpha_t}\right| \leq \frac{2(1+\gamma)\epsilon}{\sigma_m\beta}.$$ This bounds error propagation for fixed $\sigma_m$ and shows how $\beta$ controls sensitivity to prediction errors. Recomputing the batch-wide normalization can additionally affect redistribution strength. These analyses support GRAW's redistribution design: direction awareness and exponential weighting contribute to performance, while sign and budget preservation provide safeguards against inaccurate value predictions. We will include these results in the revised manuscript. We hope our responses address your concerns and welcome any further questions or suggestions.

Comments on the paper

2 comments
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Common Response

Dear Reviewers and Area Chairs,

We sincerely thank you for your time, thoughtful reviews, and constructive feedback. We are grateful that the reviewers recognized the key insights of our credit reliability analysis, the novelty and practicality of GRAW, and the strength of our empirical evaluation. Your feedback has helped us further strengthen the manuscript.

We have carefully addressed your comments and revised the manuscript accordingly. The key revisions are summarized below:

  • Robustness and generalizability of non-parametric credit analysis, including 64 MC continuations and Tree-GRPO evaluation (Appendix D).
  • Statistical analyses of performance gains, including seed-level paired tests and checkpoint-level consistency (Appendix C.2).
  • Lightweight value head reliability and stability under policy updates (Section 5.2 & Appendix C.4).
  • Clarification of progress-based evaluation and direct MC-based validation of credit redistribution (Section 5.4 & Appendix C.7).
  • Additional ablations of credit redistribution, including alternative weighting strategies and component-wise ablations (Appendix E).
  • Theoretical interpretation and robustness analysis of the redistribution mechanism (Appendix E).
  • Expanded discussion of related methods, particularly ECPO and StepOPSD (Section 6).

All revisions are highlighted in blue in the updated manuscript for ease of reference. We welcome any further questions or comments.

Best regards,
The Authors

If the authors have addressed your concerns or provided clarifications, please join the discussion to indicate whether your concerns have been resolved or if you have any further questions.

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