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Under review as a conference paper at ICLR 2027

Where Does Task Identity Live? FLAT: A Provenance-Complete Fixed-Log Audit for Offline Task Identification

Abstract

A fixed offline log may lack task-identifying evidence, hold evidence an encoder discards, or carry task identity through task-dependent collection; encoder accuracy alone cannot tell these cases apart. We introduce FLAT (Fixed-Log Audit for Task Identification), which upper-bounds passive task identification on a fixed log relative to a declared generative factorization. Each observed factor is declared COMMON, CALIBRATED, or UNKNOWN before it is sampled, and the declaration must be complete, which the log cannot verify. FLAT stops before the first UNKNOWN factor and reveals the task on stopped episodes, which keeps the bound conservative; full likelihoods, likelihood ratios, or directional KL then give an informative ceiling, a vacuous ceiling, or no number. On reward-free PointRobot logs from 100 task-specific actors, the certified identification bracket rises from at one step to at 20 steps, whereas shared-policy logs whose reward-free factors are all COMMON have the exact prior-level ceiling . Learned identifiers recover task identity from the task-specific logs even without rewards, showing that collection itself can carry usable task signal. Across 48 search configurations (640 seeded runs), the audit maps informative and vacuous certificates; reached-stop RadSearch and a controlled stochastic Walker variant stay informative under partial modeling, and, under a uniform prior, a controlled family locates most slack in directional-KL summaries. The contribution is the fixed-log provenance formulation, its conservative treatment of unmodeled mechanisms, and certificates that use exactly the information the declaration supplies.

Primary area:
reinforcement learning
Keywords:
Offline Meta-Reinforcement Learning, Task Identification, Information-Theoretic Certificates, Data Provenance, Fixed-Log Auditing, Statistical Identifiability

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Paper summary

This paper studies a task-identifying problem in meta-reinforcement learning. The authors point out that the task-identifying accuracy of encoder does not only reflect the information in the data, but also could come from leakage in data collection strategy. Therefore, the authors propose FLAT, a framework aiming to build an upper bound for task-identifying accuracy with statistical guarantee. Specifically, it divide a collected log into three parts: common, calibrated and unknown. The key idea in FLAT is to stop auditing before the first unknown factor and assume the subsequent factors can reveal the real task. The authors then provide three methods to calculate the accuracy upper bound based on different information we have when auditing. The authors further validate their claim in experiments.

Critical strengths

The authors identify the problem that task-identifying accuracy of encoder does not only reflect the information in the data, but also could come from leakage in data collection strategy. And propose a framework for auditing it.

Critical weaknesses

Since the theory part is relatively standard, I am a little bit worried about the significance of this paper. It may be hard for real data to satisfy the assumption in the paper. We may not know the mechanism generating the data.

Questions for authors
  1. Could the authors further clarify the practical significance of the proposed method? Specifically, it would be good if the authors could provide a concrete example.
3 comments

Thank you for asking for a concrete use case and for raising concerns about the significance and practical assumptions of an audit built from established information-theoretic ingredients.

Direct question

Q1. Could the authors clarify the practical significance of FLAT with a concrete example?

To illustrate the practical value of FLAT, consider a researcher evaluating a task encoder on an offline meta-RL dataset. Suppose a FOCAL-style identifier achieves an accuracy of 0.581 on reward-free PointRobot contexts. From this number alone, it is difficult to tell whether the encoder has failed to recover available task information or whether the logged data simply do not contain enough information for better identification.

FLAT helps answer this question by providing a certified reference for the best achievable identification accuracy on the same fixed contexts. In our experiments, FLAT places this limit within [0.790, 0.800], revealing at least a 20.9-percentage-point gap between the learned identifier and the information available in the log. This tells the researcher that there is substantial room to improve task identification without necessarily changing the dataset.

FLAT can also help researchers understand how data collection affects this limit. To investigate this, we added experiments comparing different checkpoint-based collection protocols on the same 100 PointRobot tasks. At H=20, the certified limit changes from [0.993, 1.000] for final actors to [0.544, 0.555] for early snapshots. Moreover, even with the same checkpoint pool and number of episodes, independently sampling checkpoints for each episode gives [0.991, 1.000], compared with [0.893, 0.911] when one checkpoint is shared across the context.

Together, these examples illustrate how FLAT can help researchers evaluate encoder limitations, quantify the information available in offline contexts, and understand the effects of collection and context-construction protocols (Section 4.2; Appendix D).

Additional weaknesses

Standard theory. We agree the Blackwell and KL/TV ingredients are established. Our contribution is the complete factor declaration, conservative stop-and-reveal audit, calibrated certificate interface, and certified comparison between a learned encoder and the best achievable identifier on a fixed log—not a new mathematical inequality about OMRL, and we did not claim any theory either.

Applicability to real-world datasets. We acknowledge that real-world offline datasets may lack the collection provenance or calibrated likelihood information needed for an informative certified upper bound. However, this does not necessarily prevent FLAT from being used as an approximate diagnostic. When exact likelihoods are unavailable, behavior cloning (BC) and world models (WM) can be fitted to task-labeled offline trajectories to estimate candidate action or transition likelihoods. These estimates can then provide potentially useful reference values for task-identification evaluation, although they are not certified upper bounds without additional model-error guarantees.

To investigate this possibility, we added experiments comparing FLAT values computed from fitted BC/WM models against exact-likelihood references (Section 4.4; Appendix G). In our controlled experiments, some fitted models produce estimates close to the exact-likelihood references, although their accuracy depends on the model and available data. For example, goal-conditioned BC trained with 1,000 episodes per task gives Real/Model values of 0.514/0.515, compared with the certified PointRobot bracket [0.509, 0.519]. On stochastic Walker, a simulator-structured WM gives 0.804/0.833 against an exact-likelihood reference near 0.810.

We also report cases where fitted models are inaccurate, particularly with limited data. Thus, the additional experiments demonstrate the potential usefulness and limitations of approximate FLAT diagnostics. They do not establish reliable certification or estimation for arbitrary real-world datasets, including human demonstrations, which remain untested.

Thank you for the clarification and examples. The explanation and experiments results are helpful. But I think the world model experiment is not enough to support the framework usefullness under unknown mechanism. The strong result depends on the world model knowing the simulation structure. Overall, I decide to keep my score.

Thank you for the follow-up. We agree. The simulator-structured result assumes a known simulator family, as stated in Appendix G.3, and our experiments do not show that learned likelihoods are reliable for unknown task-dependent dynamics.

We would like to clarify one point of scope. FLAT needs likelihoods only for factors that depend on the task. A factor whose law is the same under every candidate is declared COMMON and cancels from every comparison, so its numerical form is never needed. What is required is the qualitative fact that the factor does not depend on the task. This is usually fixed by the benchmark definition, and a wrong declaration of this kind can be detected by the diagnostic probes of Appendix C.4.

In reward-varying benchmarks such as PointRobot and HalfCheetah-Vel, the physical transition is COMMON. All certified collection-protocol results in Section 4.2 therefore use no transition model. They still require the collection-policy likelihoods, which the dataset creator holds (Table 1). The shared-policy logs reach the exact prior-level limit with no likelihood at all. Unknown task-dependent dynamics remain a limitation; dynamics that are unknown but task-invariant are not.

We also note that requiring only the simulator family, rather than the exact dynamics, already broadens where FLAT applies. Dynamics-varying OMRL benchmarks are generated from known simulators with randomized parameters, so this setting covers a large class of existing benchmarks, even though the results there are estimates rather than certificates.

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Paper summary

This paper proposes FLAT, an audit that upper-bounds, relative to a declared generative factorization, how well the task can be identified from a fixed offline log in offline meta-reinforcement learning (OMRL). The motivation is that encoder accuracy alone cannot distinguish (1) whether the log lacks task information, (2) whether the encoder discards available information, or (3) whether the data-collection policy itself injects task identity. FLAT asks the auditor to declare each generative factor of the log as COMMON, CALIBRATED, or UNKNOWN before it is sampled, stops just before the first UNKNOWN factor, and treats the true task label as revealed thereafter, which yields a conservative ceiling. Depending on whether full likelihoods, likelihood ratios, or KL bounds are available, a different certificate route is used, with one-sided finite-sample confidence endpoints. Experiments show that reward-free PointRobot logs collected by task-specific actors become almost perfectly identifying within 20 steps, whereas shared-policy logs whose reward-free factors are all COMMON stay at the prior level, demonstrating that data collection itself can carry task identity.

Critical strengths

The problem formulation, which separates encoder performance from the amount of task information contained in the log, is clear and offers an important perspective for interpreting encoder evaluations in OMRL. On the theoretical side, the simple construction of stopping at the first UNKNOWN factor and revealing the label thereafter yields an upper experiment that Blackwell-dominates the log (Theorem 1), so the ceiling remains valid even when some mechanisms are not modeled. The paper shows that completeness of the declaration is necessary for any nontrivial ceiling (Proposition 1), and its fail-closed design, which reports no number when conditions are not met, makes the scope of the guarantee explicit. The paper also certifies that reward-free logs from task-specific actors are almost fully identifying and empirically confirms that learned identifiers can exploit this signal, which is valuable evidence that high encoder accuracy can stem from the collection policy.

Critical weaknesses

First, it remains unclear how many factors would be UNKNOWN in typical fixed offline logs. The paper acknowledges that completeness of the declaration cannot be verified from the log, but a separate issue remains: data with unknown behavior policies (human demonstrations, replay buffers without saved checkpoints) or transitions without available likelihoods render factors UNKNOWN. Indeed, in the paper's own Walker2d example, the audit stops at the first transition and the ceiling is one. In the search-domain factorial, none of the 341 informative cells had any context reaching the selected neighborhood, and the cases that remain informative after reaching UNKNOWN (RadSearch and the stochastic Walker variant) were obtained with settings chosen after pilot experiments.

Second, while the introduction strongly motivates the work with encoder evaluation in OMRL, informative ceilings, apart from the prior-level shared-policy case, are obtained only in simulations whose generative processes are known by construction, and applicability to real data is not sufficiently discussed. The data-collection protocol also differs from common practice (replay buffers or mixtures of checkpoints), and the reason is not given. Explicitly discussing what data creators should record as audit metadata, separate from the context given to identifiers (behavior policies, checkpoints, episode-to-policy correspondence, etc.), would substantially increase the practical value of the work.

Questions for authors
  1. Applicability to conventional OMRL data: Many prior OMRL studies use per-task replay buffers or trajectories collected by multiple training checkpoints, whereas this paper newly collects data with a single frozen actor per task. Why was this collection protocol chosen? What would need to be recorded for auditing in order to apply FLAT to conventional data, and for existing data without such records, would the action factor become UNKNOWN and the ceiling equal one?

  2. Data whose behavior policy is fundamentally unknown: What can FLAT say about data such as human demonstrations, where behavior-policy likelihoods are unavailable? Apart from the shared-policy case, is there any way to obtain an informative ceiling? How many factors do the authors expect to be UNKNOWN in realistic logs, given that all informative search-domain results correspond to cases where no context reached the stop?

  3. Positioning of FLAT: Is FLAT intended as a tool to be applied directly to encoder evaluation in practical OMRL, or as a framework for demonstrating phenomena under controlled conditions? If the latter, we suggest revising how the motivation is presented in the introduction. If the former, we would like to see applications to the kinds of data used in prior work, i.e., data collected under conventional protocols.

2 comments

Thank you for the thoughtful questions about conventional collection, missing provenance, and UNKNOWN factors.

Q1. Conventional collection and missing provenance

We initially used one frozen SAC actor per task to establish a controlled reference with exactly evaluable collection likelihoods, rather than because FLAT requires a single stationary collector. To address the concern about conventional OMRL data collection, we added experiments with separately trained final actors, early and late training snapshots, and replay-buffer-style checkpoint mixtures, evaluated on the same 100 PointRobot tasks. For example, at (H=20), the certified identification bracket changes from [0.993, 1.000] for final actors to [0.790, 0.800] for buffer-style mixtures. Furthermore, changing how checkpoints are sampled across episodes within a context also changes the identification limit (Section 4.2; Appendix D).

Regarding what needs to be recorded, we added a practical provenance checklist in Table 1 (Section 3.1). It specifies the candidate tasks and prior, observed fields, collection protocol, factor declarations, and the likelihood information required by different audit routes. For checkpoint mixtures, both mixture probabilities and checkpoint-sampling rules are important. However, retaining the original policy checkpoints is not always necessary: on PointRobot, a stored candidate log-likelihood table of approximately 480 MB reproduces the certificate without them (Appendix E.3).

When the required likelihood information cannot be recovered or independently calibrated, the corresponding task-dependent mechanism must be treated as UNKNOWN. If this occurs before any useful task information is observed, FLAT may return a vacuous upper bound of one. For example, in our buffer-style PointRobot audit at H=20, the upper endpoint increases from 0.800 with known collection provenance to 1.000 when the collector mixture is only known to belong to four specified alternatives, or when the behavior policy is UNKNOWN (Appendix E.3, Table 21). However, we also investigated practical alternatives based on behavior cloning (BC) and world models (WM) fitted from offline trajectories. Although their likelihood estimates do not provide certified upper bounds without independent error guarantees, they can yield useful approximate references for evaluating task identifiability, as demonstrated in Section 4.4 and Appendix G.

Q2. Human demonstrations and reached UNKNOWN

FLAT cannot generally provide an informative certified upper bound when a task-dependent behavior policy is entirely unknown and no useful calibrated information precedes it, as may occur with human demonstrations. However, behavior cloning (BC) can be fitted to task-labeled demonstrations to estimate the candidate action likelihoods, potentially providing a useful approximate FLAT reference for task-identification evaluation. Such estimates are not certified upper bounds without additional model-error guarantees, and their reliability on human demonstrations remains to be evaluated.

Importantly, encountering an UNKNOWN factor does not necessarily make a certificate vacuous: FLAT can retain task information accumulated before that factor and conservatively reveal the task afterward.

We acknowledge that none of the 341 informative runs in the initial search-domain factorial reached UNKNOWN, and that the focused reached-stop settings were pilot-informed. The original random-parameter Walker experiment also illustrates a failure case: the first uncalibrated transition is UNKNOWN, leaving a vacuous ceiling of one (Appendix D.4, Table 16). To examine whether informative certificates can still be obtained when UNKNOWN is actually encountered, we added systematic RadSearch and stochastic Walker experiments, each covering 300 runs across 30 configurations and ten seeds.

In RadSearch, 161/300 runs yield informative ceilings, including 20 that reach UNKNOWN. In stochastic Walker, all 300 runs reach UNKNOWN in at least one episode, but only 78 yield informative ceilings; the remaining 222 are vacuous, with 153 due to identification saturation and 69 due to UNKNOWN. We also added a focused Walker confirmation experiment in which 16.7–19.5% of episodes reach the unmodeled regime; all ten confirmation seeds yield informative ceilings of [0.832, 0.847] across seeds (Sections 4.1 and 4.3; Appendices C.6 and D.4).

These findings demonstrate that stopping-and-revealing can remain informative when UNKNOWN occurs, rather than only when it is avoided. Nevertheless, informativeness is not guaranteed: many settings remain vacuous, and the RadSearch certificates can still be loose (median ceiling-minus-oracle gap 0.509), whereas the corresponding median gap in Walker is 0.044.

Q3. Is FLAT a practical OMRL encoder-evaluation tool or mainly a controlled demonstration?

Our primary goal is to develop FLAT as a tool for evaluating OMRL task encoders against the information available in their offline contexts. Instead of assessing an encoder only through its identification accuracy, FLAT provides a reference for what any identifier could achieve from the same logged information.

Under documented or reconstructible collection provenance and suitable calibration, this reference is a certified identification limit. This makes FLAT most directly useful for datasets with documented or reconstructible collection processes, including controlled OMRL benchmarks. We have not yet demonstrated certified auditing on uninstrumented real-world logs. The additional checkpoint-based collection experiments discussed in Q1 demonstrate its use beyond a single frozen-actor protocol, while the provenance checklist provides concrete guidance for dataset creators.

For existing datasets where exact behavior-policy or transition likelihoods are unavailable, fitted behavior cloning or world models can instead produce approximate identification references. As shown in our additional experiments, these estimates can be close to exact-likelihood references with sufficient fitting data and appropriate model structure, although they do not retain certification guarantees.

Thus, FLAT is intended as a provenance-aware OMRL encoder-evaluation tool, with certified auditing under suitable information assumptions and approximate diagnostics when likelihoods must be learned.

Additional weaknesses

Selection bias and scope of confirmation. To address concerns about pilot-selected settings, we added systematic UNKNOWN grids specified before evaluating their outcomes, reporting both informative and vacuous cases rather than only favorable examples. We also clarified the distinction between pilot-informed experiments, systematic evaluations, and independent confirmation. For estimated-likelihood experiments, Appendix G.3 documents separate fitting, validation, and confirmation data, including the model-class-aware convergence criterion amended after fitting but before confirmation. Checkpoint-mixture BC and HalfCheetah likelihood-fitting extensions are explicitly identified as exploratory.

Representation evidence and presentation. We also highlight an existing result from Appendix F comparing task information in raw contexts and learned representations. In Appendix F, a CTMRL diagnostic achieves 0.875 task-identification accuracy from raw contexts but only 0.349 from the learned embeddings. Together with the FOCAL-style identifier comparison against certified limits in Table 3, this provides evidence that learned representations can fail to retain task information already available in the logged data. These are task-identification diagnostics, not claims of improved downstream control performance.

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Paper summary

The main contribution from this paper is an audit of how much task information is available in the offline trajectories (logs), and the primary relevance is bridging the information in the logs and what an encoder can recover from it. FLAT has the user describe how the log was generated with three labels- which mechanisms used across tasks, which have task-dependent likelihoods, and which are unknown (in which case the audit assumes perfect task identification from that point for a conservative upper bound). In PointRobot, task-specific collection makes reward-free trajectories almost perfectly identified after 20 steps compared with shared-policy collection at chance. They also test partial modeling in search environments and a controlled Walker setting. Therefore, I would say the main contribution is a framework for organizing these assumptions about how the data were collected and combining them with existing statistical bounds.

Critical strengths

The authors handle unknown mechanisms sensibly with clear explanations. Specifically, they control whether an audit can overlook info that could invalidate its bound by stopping before an unknown factor. The paper also does confine the assumptions the user must supply. The controlled experiments do show the bounds can be helpful. The Walker example also gives some useful bounds when some episodes reach an unknown regime.

Critical weaknesses
  • The main weakness is that the theoretical claims are limited. The main upper bound compares the observation process with the original log and some established information bounds (i.e. Theorem 1). But I don’t see a new result about task inference beyond that. The audit also requires a complete account of the logging process and justified likelihoods or divergence bounds so much of the usefulness depends on information supplied outside the log.
  • The impact of the experiments are also limited by how much info is built into the settings. PointRobot gives the likelihoods of the candidate actors and the upper-bound calculation uses stored generation latents. The Walker example is similar with full-state logging, known transition noise, and a narrower task-parameter range.
Questions for authors
  • What’s the main new task-inference conclusion that’s beyond the known effects of the collection policy + existing information bounds?
  • How useful are the certificates when we need to estimate the collection policy and transition likelihoods from data?
2 comments

Thank you for recognizing the value of the provenance-aware audit and its conservative treatment of unmodeled mechanisms. We agree that the individual information-theoretic tools are established, and have clarified the scope of our contribution and expanded the experiments.

Direct questions

Q1. What new task-inference conclusion goes beyond known collection-policy effects and existing information bounds?

We agree that the underlying Blackwell/KL/TV bounds and the observation that task-dependent collection policies can reveal task identity are not new. Our contribution is to turn these established tools into a systematic audit of task information in fixed offline logs, explicitly accounting for how the data were collected and conservatively handling mechanisms that cannot be modeled. Under the required provenance and calibration assumptions, FLAT provides a certified quantitative limit on task identification. This enables conclusions that neither encoder accuracy alone nor the known qualitative leakage effect can provides, which is a major contribution.

First, it distinguishes information limitations from encoder limitations. A low encoder accuracy may reflect insufficient task information in the log or information that the encoder fails to recover. For example, on buffer-style PointRobot logs, a FOCAL-style identifier achieves 0.581 accuracy, while FLAT certifies an optimal identification accuracy within [0.790, 0.800], revealing at least a 20.9% gap.

Second, FLAT quantifies how the information limit depends on collection and context-construction protocols. To investigate this, we added experiments comparing final task-specific SAC actors, early and late training snapshots, replay-buffer-style checkpoint mixtures, and shared-actor collection on the same 100 PointRobot tasks. At H=20, the certified brackets range from [0.993, 1.000] for final actors to [0.544, 0.555] for early snapshots, while shared-actor collection has an exact prior-level limit of 0.010.

Moreover, even with the same checkpoint pool and number of episodes, how episodes are grouped into contexts changes the limit: independently sampling checkpoints per episode yields [0.991, 1.000], compared with [0.893, 0.911] when one checkpoint is shared across the context.

These results show that FLAT goes beyond detecting collection-policy leakage: it quantifies the available task information, identifies encoder headroom, and reveals how collection and context construction determine the identification limit (Section 4.2; Appendix D).

Q2. How useful are certificates when collection-policy and transition likelihoods must be estimated from data?

Fitted likelihoods do not, by themselves, yield certified true-process upper bounds. However, they can provide useful approximate reference values for task-identification diagnostics when exact policy or transition likelihoods are unavailable. We added held-out Behavior cloning (BC)/ World Model (WM) evaluations against exact-likelihood references, separating Real (maximum fitted posterior on actual held-out logs) from Model (Bayes identification accuracy under the fitted generative law), and reporting a held-out lower confidence bound on the fitted identifier's accuracy (Section 4.4; Appendix G).

With sufficient fitting data and suitable model structures, the approximate values can be close. For PointRobot final-actor logs at H=8, goal-conditioned BC fitted with 1,000 episodes per task gives Real/Model values of 0.514/0.515, compared with the exact bracket [0.509, 0.519]. In stochastic Walker, simulator-structured estimation of both physical parameters and noise gives 0.804/0.833 against an exact-reference point estimate near 0.810. We further examined whether this close agreement in the overall FLAT estimate also holds at the posterior level. Across five BC seeds, the fitted and exact task posteriors have a mean total-variation distance of 0.047 ± 0.008, and their most likely tasks differ on 8.0 ± 1.6% of held-out episodes (mean ± SD). Thus, the close agreement in the aggregate estimate does not necessarily imply equally close agreement between individual task posteriors.

We also report failure cases: with only 10 PointRobot fitting episodes, Gaussian BC gives a Model estimate of 0.456, below the true-reference lower endpoint 0.509; a shared neural Walker model produces a nominal upper of 0.737, below the true-reference lower endpoint 0.742.

These results show when fitted models are informative approximate diagnostics, while confirming that independent model-error guarantees are needed before treating them as certified upper bounds. The simulator-structured Walker result assumes a known simulator family.

Additional weaknesses

Completeness of provenance. We agree that the completeness of the declared generative factors cannot be verified from the fixed log alone. We now make this assumption explicit and provide a checklist of the required information in Table 1. If an observed task-dependent factor is omitted from the declaration, the resulting certificate will not be justified and the audit must refuse rather than report an unsupported bound.

Privileged action-generation latents. To check whether the reported PointRobot brackets depend on privileged action-generation latents, we added an independent computation using exact probabilities of the recorded float32 action cells. The resulting identification brackets agree with the latent-augmented calculation to four decimal places across all six audited horizons. Appendix D.1 now documents this verification and the precise information available to the auditor and identifier.

Walker calibration and task-range sensitivity. We added a sensitivity experiment varying Walker task-parameter spread over five levels (60 runs per level) and clarified the information assumptions of the simulator-structured WM (Appendix D.4 and Appendix G). At the two widest spreads, all 120 runs already have certified identification lower bounds of at least 0.95, so vacuous upper endpoints can reflect near-saturated identifiability rather than only failure of the stopping method. The informative counts at spreads 0.25, 0.5, and 1 are 40/60, 30/60, and 8/60.

The fitted simulator-structured WM estimates both physical parameters and noise rather than receiving their true values. We still explicitly acknowledge that this study uses full simulator state and a known noisy-simulator family.

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