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Under review as a conference paper at ICLR 2027

Terminal-World: Scaling Terminal Agent Environments via Agent Skills

Abstract

Terminal agents enable Large Language Models (LLMs) to flexibly compose command line actions, extending their action space to achieve superior generalizability. To train such agents, existing methods construct training data by first fixing one of the three required components (i.e., a task instruction, an executable environment, and an expert trajectory), such as tasks from seed keywords or environments from GitHub repositories, and then completing the rest around it. However, such pipelines synthesize the three components in isolation, making it difficult to maintain coherence among the three as data scales, limiting the effectiveness of data scaling for agent improvement. To mitigate this, we introduce Terminal-World, a unified framework that uses agent skills as its core primitive to automatically synthesize coherent training data at scale. Specifically, each skill naturally encodes what to accomplish, when to apply it, and how to execute it, enabling the task, environment, and trajectory to be jointly derived from a single specification rather than assembled independently. With this framework, we construct the dataset Terminal-Atlas and train Terminal-Navigator-8B/14B/32B. Using the same teacher and base model with only 1.2% of the training data, Terminal-Navigator-32B achieves 31.5 vs. 27.0 Pass@1 and 43.8 vs. 37.1 Pass@3 on Terminal-Bench 2.0. These results highlight Terminal-World's ability to efficiently synthesize high quality training data.

Primary area:
datasets and benchmarks
Keywords:
terminal agent, agent skill, data synthesis, multi-agent, coding agent

Reviews

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1234this paper, Top 32%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.50 over 4 reviews, above 68% of the others.
Reviewer_qJSWOpenReview ↗
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3
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3
Informativeness
2
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2
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Paper summary

Terminal-World constructs terminal-agent training data from existing agent skills. It pairs filtered skills with personas to generate instructions, environment blueprints, evaluation criteria, and execution guidelines. A generate–verify–repair pipeline builds files, setup scripts, and pytest verifiers, after which a guided teacher collects trajectories. Guidelines are removed from student training inputs, and both successful and failed trajectories are retained. The resulting Terminal-Atlas contains 5,723 tasks from 1,000 skills. SFT produces Terminal-Navigator models at 8B, 14B, and 32B. The 32B model obtains 31.5% Pass@1 on Terminal-Bench 2.0 versus 27.0% for the evaluated Nemotron-Terminal-32B baseline. The paper also evaluates five terminalized benchmarks, training-data ablations, SFT followed by GRPO, environment quality, and synthesis cost.

Critical strengths
  1. The dataset demonstrates substantial training utility with a compact number of trajectories. Table 3 evaluates three model sizes across six benchmarks, and the 32B model is competitive with a substantially larger training dataset under a common local inference configuration (Appendix B.3). The 5,723/490,520 trajectory ratio is approximately 1.17%, consistent with the rounded 1.2% claim. Regardless of whether this isolates the cause of efficiency, the observed downstream performance makes the proposed data source practically interesting.

  2. Several design choices receive targeted empirical support. Appendix C.5 compares guided and unguided teacher collection on the same 500 tasks, reporting success of 39.6% versus 27.6%. Table 4 separately tests retaining guidance during SFT and compares a reduced dataset against success-only training at the same approximate size. The paper also includes multiple judges and human checks for task-quality filtering and two downstream evaluation benchmarks. This is more informative than presenting an automated pipeline without investigating its supervision choices.

Critical weaknesses
  1. The reliability of the generated verification signal remains unresolved, including a concrete false-positive path in the displayed code. In Appendix E.2, p.42, test_conflicts_json_content checks that a list exists and validates entries only if present. The object {"total_conflicts": 0, "conflicts": []} therefore passes this function despite the explicitly documented conflict for student 101. The function does not require that conflict to appear or validate the conflict count. This is a bounded defect in the shown example, not evidence that all dataset verifiers are wrong. Nevertheless, merely failing on the initial state (§3.3) cannot exclude such incomplete-output passes. In the opposite direction, Appendix C.2 reports that LLM judges consider 67.7% of 300 verifier-failed trajectories complete. Without adjudication using task requirements and final artifacts, this could reflect verifier false negatives or judge leniency. It weakens both the reliability claim and the interpretation of low teacher success as evidence of task difficulty, particularly when the same environments supply RL rewards.

  2. The central explanation of data efficiency is not isolated. Sharing the teacher and base model does not control training tokens, optimization, filtering, task mix, or the contribution of skill-derived guidance. Table 4 studies within-pipeline choices but does not compare joint versus separately constructed specifications under an otherwise matched recipe. Nor is there a matched-size or matched-token comparison with the competing training data. Thus, the 1.2% ratio establishes a trajectory-count comparison, not an 83-fold compute advantage or proof that coherence is the cause. The broad description of prior synthesis as isolated also needs refinement: the already cited Nemotron-Terminal paper includes primitive-skill generation and a common task/test/input/environment format (§§4.2.2–4.2.3). The distinction should focus on the specific use of reusable workflow packages and their measured contribution. Pi et al., original paper.

Questions for authors
  1. Clarification and limited verifier audit: Does the released verifier include an additional check absent from p.42 that rejects an empty conflict list? Can a small artifact-level audit distinguish real task failures, verifier errors, and judge errors in the 300-case sample, and test known-correct solutions plus deliberately incomplete outputs? This would directly affect my assessment of the environments and RL results.
  2. Limited validation of the mechanism: Can one controlled training comparison, for example at 8B, hold the teacher, training budget, filtering, and approximate token count fixed while changing joint skill-based specification or using a matched subset of baseline data? This would help determine whether the benefit is attributable to the proposed construction principle.
  3. Clarification of uncertainty and data independence: How are Pass@3 and its standard error computed from the reported three runs, and what is the paired task-level uncertainty for the 31.5% versus 27.0% comparison? Beyond the stated Terminal-Bench 14-gram filter, what overlap checks were applied to the collected skills and the other evaluation benchmarks?
6 comments
AuthorsOpenReview ↗

Response to Reviewer qJSW (1/5)

We sincerely thank the reviewer for the careful and constructive feedback. We appreciate your recognition of our dataset's training utility with relatively few trajectories and the empirical support for our design choices. Following your suggestions, we have added verifier checks and controlled comparisons, and clarified the evaluation protocol and data overlap checks. We address each concern below.


W1: The reliability of the generated verification signal remains unresolved, including a concrete false-positive path in the displayed code. In Appendix E.2, p.42, test_conflicts_json_content checks that a list exists and validates entries only if present. The object {"total_conflicts": 0, "conflicts": []} therefore passes this function despite the explicitly documented conflict for student 101. The function does not require that conflict to appear or validate the conflict count. This is a bounded defect in the shown example, not evidence that all dataset verifiers are wrong. Nevertheless, merely failing on the initial state (§3.3) cannot exclude such incomplete-output passes. In the opposite direction, Appendix C.2 reports that LLM judges consider 67.7% of 300 verifier-failed trajectories complete. Without adjudication using task requirements and final artifacts, this could reflect verifier false negatives or judge leniency. It weakens both the reliability claim and the interpretation of low teacher success as evidence of task difficulty, particularly when the same environments supply RL rewards.

Q1: Clarification and limited verifier audit: Does the released verifier include an additional check absent from p.42 that rejects an empty conflict list? Can a small artifact-level audit distinguish real task failures, verifier errors, and judge errors in the 300-case sample, and test known-correct solutions plus deliberately incomplete outputs? This would directly affect my assessment of the environments and RL results.

Thank you for identifying this issue. We manually inspected this task's SFT trajectories and Qwen3-8B/14B RL rollouts and found no false positives caused by the empty-conflict-list loophole.

Our synthesis pipeline includes checks of both task specifications and executable environments. Following your suggestion, we added three experiments to assess verifier reliability. We present the existing quality controls and new quantitative evidence below.

  • (1) Qualitative measures.

    • (1.1) Joint synthesis and cross-model filtering. As stated in lines 208-215, we jointly generate task instructions, environment blueprints, and evaluation criteria, then apply LLM-based quality filtering. DeepSeek-V3.2 generates the specifications; Gemini-3.5-Flash judges them and constructs the environments. The filter explicitly checks Evaluation Criteria Quality, including whether completion conditions are clear and can be translated into reliable pytest checks (Appendix D.3, lines 1519-1527). We retain only specifications scoring at least 4 out of 5 on every dimension.

    • (1.2) Execution checks and repair. As stated in lines 248-260, we check initial-file correctness, cross-file consistency, dependencies, and runtime states. We also verify that the tests execute correctly and reject the initial state. Detected issues trigger repairs, and tasks that remain invalid after three iterations are discarded (lines 236-244).

  • (2) Quantitative evidence. We independently reviewed verifier decisions, tested deliberately incorrect outputs and task solvability, and re-examined the 300 failed trajectories in Appendix C.2.

    • (2.1) Reviewing verifier decisions. We sampled 50 verifier-passed and 50 verifier-failed trajectories. Codex with GPT-6-Astra (medium effort) independently checked their final artifacts against the task requirements.

      Verifier decisionCountAgreement (%)
      Pass44/5088
      Fail46/5092

      The review supported most acceptance and rejection decisions in this sample.

    • (2.2) Testing modified outputs and solving failed tasks. Using the same samples, we asked Codex with GPT-6-Astra to introduce one explicit requirement violation into each verifier-passed output, then reran the verifier. For each originally failed task, the model made three independent attempts from the initial environment. We independently checked the resulting artifacts before counting successes.

      TestCountRate (%)
      Modified outputs rejected48/5096
      Tasks solved within three attempts45/5090

      The verifier rejected 96% of deliberately flawed outputs, while the successful retries confirmed that at least 90% of the sampled tasks were solvable despite the original teacher failures.

AuthorsOpenReview ↗

Response to Reviewer qJSW (2/5)

Continued response to W1/Q1: re-examining the 300 verifier-rejected trajectories.

  • (2.3) Re-examining the 300 rejected trajectories. We manually checked their final artifacts against the task requirements and reproduced the failed checks to distinguish genuine task failures from verifier errors.

    Original LLM verdictGenuine task failuresVerifier false rejections
    Complete181/203 (89.2%)22/203 (10.8%)
    Incomplete96/97 (99.0%)1/97 (1.0%)
    Overall277/300 (92.3%)23/300 (7.7%)

    Of the 203 trajectories originally judged complete, 181 (89.2%) violated explicit task requirements. This explains the discrepancy: the original trajectory-based LLM judges overestimated completion, while the final artifacts support most verifier rejections.

Overall, these checks support most verifier decisions in the reviewed samples and show that most audited teacher failures involved unmet requirements. Table 6 further shows that adding GRPO after SFT improves Terminal-Bench 2.0 Pass@1 by 2.25 percentage points at both 8B and 14B, supporting the environments' utility for RL training.

AuthorsOpenReview ↗

Response to Reviewer qJSW (3/5)

W2: The central explanation of data efficiency is not isolated. Sharing the teacher and base model does not control training tokens, optimization, filtering, task mix, or the contribution of skill-derived guidance. Table 4 studies within-pipeline choices but does not compare joint versus separately constructed specifications under an otherwise matched recipe. Nor is there a matched-size or matched-token comparison with the competing training data. Thus, the 1.2% ratio establishes a trajectory-count comparison, not an 83-fold compute advantage or proof that coherence is the cause. The broad description of prior synthesis as isolated also needs refinement: the already cited Nemotron-Terminal paper includes primitive-skill generation and a common task/test/input/environment format (§§4.2.2–4.2.3). The distinction should focus on the specific use of reusable workflow packages and their measured contribution. Pi et al., original paper (https://arxiv.org/html/2602.21193v1).

Q2: Limited validation of the mechanism: Can one controlled training comparison, for example at 8B, hold the teacher, training budget, filtering, and approximate token count fixed while changing joint skill-based specification or using a matched subset of baseline data? This would help determine whether the benefit is attributable to the proposed construction principle.

Thank you for these suggestions. Following your recommendation, we conducted a controlled synthesis ablation and trained two Nemotron-Terminal-8B baselines with matched budgets. Unified synthesis improves task-environment consistency and downstream performance, and our data-efficiency advantage persists under matched trajectory and token budgets.

  • (1) Contribution of unified synthesis. We compare unified and isolated synthesis using the same agent skills, synthesis models, environment construction and verification pipeline, and teacher settings. In isolated synthesis, we first generate the task instruction and then derive the environment blueprint from that instruction alone. Both settings use 2.3K trajectories to fine-tune Qwen3-8B with identical SFT hyperparameters; inference follows Table 14.

    SynthesisEnvironment-task consistencyTB2.0 Pass@1 (%)TB2.0 Pass@3 (%)
    Isolated synthesis2.548.9914.61
    Unified synthesis2.9712.3617.98

    With the same skill source and trajectory count, unified synthesis produces more consistent task-environment pairs and more effective training data.

  • (2) Matched training budgets. The reported 1.2% compares 5,723 with 490,520 training trajectories. To evaluate efficiency under matched budgets, we additionally trained two Nemotron-Terminal-8B baselines matching our trajectory count and training-token budget, respectively, using the same SFT and inference settings.

    ModelTrajectoriesTraining tokens (M)TB2.0 Pass@1 (%)
    Nemotron-Terminal-8B (matched trajectories)5,72397.867.87
    Nemotron-Terminal-8B (matched tokens)13,421229.508.99
    Terminal-Navigator-8B (Ours)5,723229.4915.73

    Our model exceeds the trajectory-matched and token-matched baselines by 7.87 and 6.74 percentage points, respectively, supporting greater training-data efficiency under both budgets.

    We have added both comparisons to secs. 5.2 and 5.5 (Tables 5 and 9), with the accompanying discussion marked in blue.

  • (3) Contribution of execution guidelines. Using agent skills as a unified primitive is one of our core contributions. Their procedural knowledge supports task and environment synthesis while guiding efficient teacher trajectory collection. Appendix C.5 (Table 20) measures this guidance effect: guidelines increase teacher success from 27.6% to 39.6% and reduce average steps on successful trajectories from 14.27 to 12.66. As described in sec. 3.4, we remove execution guidelines from the student SFT inputs before training.

Reviewer_npuaOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper proposes Terminal-World, a framework for synthesizing terminal-agent training data using agent skills as unified specifications for task instructions, executable environments, and expert trajectories. The authors construct Terminal-Atlas with 5.7K trajectories and train Terminal-Navigator models at 8B, 14B, and 32B scales. The resulting models achieve competitive performance across six benchmarks using substantially fewer training trajectories than existing approaches.

Critical strengths
  • Practical and well-motivated approach. Using existing agent skills to jointly construct tasks, environments, and trajectories is a promising direction for scalable agent training.

  • The framework integrates skill collection, persona-based task generation, executable environment construction, automatic verification, and guided trajectory collection.

  • The models achieve substantial improvements over their base models, with competitive performance against methods trained on considerably more data.

  • The paper includes studies of execution guidance, data diversity, unsuccessful trajectories, environment quality, and SFT/RL complementarity.

Critical weaknesses
  • Insufficient validation of the core methodological contribution. The paper attributes its effectiveness to jointly deriving tasks, environments, and trajectories from agent skills. However, there is no sufficiently controlled comparison against conventional task-generation pipelines using the same teacher, data budget, environment construction, and training settings. Consequently, the contribution of unified skill grounding remains unclear.

  • The comparison with Nemotron-Terminal emphasizes using only 1.2% as many trajectories, but does not provide matched-budget learning curves or comparisons under equivalent token and computational budgets. The gains may also depend on additional supervision from skill-derived execution guidelines.

  • Appendix C.2 reports that 67.7% of verifier-failed trajectories are judged semantically complete by an LLM ensemble. While this may indicate that unsuccessful trajectories contain useful intermediate actions, it also raises questions about false negatives in the generated verifiers. Independent validation of these discrepancies would strengthen the reliability claims.

Questions for authors

Please refer to weakness section.

4 comments
AuthorsOpenReview ↗

Response to Reviewer npua (1/3)

We sincerely thank the reviewer for the constructive and encouraging feedback. We appreciate your recognition of our approach’s practical motivation and potential for scalable agent training, as well as our models’ competitive performance with substantially fewer training trajectories. Your suggestions on controlled comparisons, matched training budgets, and verifier reliability have helped us strengthen our evaluation. Below, we address each concern.


W1: Insufficient validation of the core methodological contribution. The paper attributes its effectiveness to jointly deriving tasks, environments, and trajectories from agent skills. However, there is no sufficiently controlled comparison against conventional task-generation pipelines using the same teacher, data budget, environment construction, and training settings. Consequently, the contribution of unified skill grounding remains unclear.

Thank you for this valuable suggestion. Following your suggestion, we conducted a controlled ablation and found that unified synthesis improves both environment–task consistency and downstream performance.

  • (1) Setting. We compare unified and isolated synthesis using the same agent skills, synthesis models, environment construction and verification pipeline, and teacher settings, with matched trajectory counts and training settings. In isolated synthesis, we first generate the task instruction and then derive the environment blueprint from that instruction alone.

  • (2) Result. Unified synthesis improves environment–task consistency by 0.43 points and TB2.0 Pass@1 and Pass@3 by 3.37 percentage points each.

    Synthesis StrategyEnv–Task Consistency ↑TB2.0 Pass@1 (%) ↑TB2.0 Pass@3 (%) ↑
    Isolated Synthesis2.548.9914.61
    Unified Synthesis (Ours)2.9712.3617.98

    These results demonstrate that unified synthesis turns the same agent skills into more coherent task–environment pairs and more effective training data, improving downstream performance with the same number of training trajectories.

    We have added this ablation to sec. 5.2 (Table 5, page 8), with the accompanying discussion marked in blue.

AuthorsOpenReview ↗

Response to Reviewer npua (2/3)

W2: The comparison with Nemotron-Terminal emphasizes using only 1.2% as many trajectories, but does not provide matched-budget learning curves or comparisons under equivalent token and computational budgets. The gains may also depend on additional supervision from skill-derived execution guidelines.

Thank you for this valuable suggestion. We address matched training budgets and the contribution of execution guidelines below.

  • (1) Matched training budgets and generalization. Following your suggestion, we additionally trained two Nemotron-Terminal-8B baselines matching our 5,723 training trajectories and 229.49M training tokens, respectively. We evaluated generalization across Terminal-Bench 1.0, 2.0, and 2.1, as well as AIME24/25, TableBench, DABench, and BIRD, following the inference settings in Table 14. Scores are Pass@1 (%).

    ModelAvg.TB Avg.Non-TB Avg.TB1.0TB2.0TB2.1AIME24/25TableBenchDABenchBIRD
    Nemotron-Terminal-8B (full)48.717.367.525.0013.4813.4873.3366.580.544.00
    Nemotron-Terminal-8B (matched trajectories)38.09.055.411.257.877.8765.0039.561.546.00
    Nemotron-Terminal-8B (matched tokens)39.411.855.917.508.998.9970.0041.052.546.00
    Terminal-Navigator-8B (Ours)52.919.273.026.2515.7315.7383.3369.580.548.50

    Terminal-Navigator-8B achieves an overall average of 52.9, compared with 38.0 and 39.4 for the trajectory-matched and token-matched Nemotron baselines, respectively. It also outperforms the full-data Nemotron-Terminal-8B [1], which achieves 48.7 overall, by 1.9 and 5.5 percentage points in TB and non-TB averages, despite the latter using 85.7× as many trajectories and approximately 36.6× as many training tokens. These results support the data efficiency and cross-domain transfer of the Terminal-World pipeline.

    We have included these comparisons and scaling curves in sec. 5.5 (Table 9 and Figure 6, page 10), with the accompanying discussion marked in blue.

  • (2) Contribution of execution guidelines. Using agent skills as a unified primitive is one of our core contributions. Their procedural knowledge supports the unified generation of task instructions, environment blueprints, and execution guidelines, enabling more efficient teacher trajectory collection. Futhermore, Appendix C.5 (Table 20) shows that guidelines increase teacher success from 27.6% to 39.6% and reduce average steps on successful trajectories from 14.27 to 12.66. Importantly, as stated in Sec. 3.4, these guidelines are used only during teacher trajectory collection and are removed from the student SFT inputs before training.

[1] Pi et al. On Data Engineering for Scaling LLM Terminal Capabilities.

AuthorsOpenReview ↗

Response to Reviewer npua (3/3)

W3: Appendix C.2 reports that 67.7% of verifier-failed trajectories are judged semantically complete by an LLM ensemble. While this may indicate that unsuccessful trajectories contain useful intermediate actions, it also raises questions about false negatives in the generated verifiers. Independent validation of these discrepancies would strengthen the reliability claims.

Thank you for raising this important concern. Following your suggestion, we independently reviewed all 300 verifier-rejected trajectories in Appendix C.2, manually checking their final artifacts against the original task requirements. Our review confirms that most disputed verifier rejections were correct: the disagreement primarily reflects the LLM ensemble overestimating task completion.

  • (1) Independent validation. Among the 203 trajectories (67.7%) judged complete by the LLM ensemble, 181 (89.2%) violated explicit task requirements. Across all 300 rejected trajectories, 277 (92.3%) were genuine task failures, while 23 (7.7%) were verifier false rejections. Independent examination of the final artifacts therefore supports the verifier’s decisions in most of the disputed cases.

  • (2) Explaining the disagreement. Trajectory-based judges can mistake plausible progress for task completion. For illustration, we present a concrete model-training case in which the task requires test accuracy above 95%. Normal training logs and a converging loss can lead an LLM judge to mark the task complete. If evaluating the saved checkpoint on the specified test set reveals accuracy below 95%, the verifier correctly rejects it. The final evaluation checks the required outcome directly, which the training logs alone cannot establish.

These findings also clarify the interpretation of Appendix C.2: a trajectory can contain useful intermediate reasoning and tool-use actions while failing the final task requirements. Table 4 shows that retaining verifier-rejected trajectories improves downstream performance, supporting their training value alongside the independent evidence for verifier reliability.


Thank you again for the constructive suggestions. We sincerely hope these clarifications and additional experiments address your concerns, and we respectfully ask you to reconsider your score.

AuthorsOpenReview ↗

A Kind Reminder for Reading the Response

Dear Reviewer npua,

Thank you again for your valuable feedback on our paper. We wanted to kindly follow up to check whether our rebuttal has adequately addressed your concerns. If any aspect remains unclear or requires further elaboration, we would be happy to provide additional clarification.

We sincerely appreciate your time and look forward to hearing from you.

Best wishes,

The Authors

Reviewer_wgDuOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

The paper introduces Terminal-World, a framework that uses agent skills as a shared source for synthesizing task instructions, executable environments, and teacher trajectories. It constructs Terminal-Atlas with 5,723 trajectories derived from 1,000 selected skills and trains Terminal-Navigator models at three sizes. Evaluation across six benchmarks shows competitive performance with substantially fewer training trajectories than the principal baseline. Additional experiments examine SFT data strategies, environment quality, generation costs, and the use of synthesized environments for RL.

Critical strengths
  1. Strong sample efficiency. Using 5.7K trajectories versus Nemotron-Terminal’s 490.5K, Terminal-Navigator-32B achieves 31.5 versus 27.0 Pass@1 on Terminal-Bench 2.0 with the same teacher and base model.

  2. Useful training environments. The framework generates executable, verifiable environments at modest reported API cost. Further gains from GRPO support their value beyond SFT data collection.

Critical weaknesses
  1. Insufficient validation of the isolation claim. Table 6 compares different datasets but does not isolate whether unified synthesis improves task–environment consistency over isolated synthesis.

  2. Limited evidence for scalability. The pipeline produces 5.7K environments, while Table 4 varies training-set size rather than synthesis scale. It remains unclear whether environment quality, construction yield, and unit cost are maintained as generation volume increases.

  3. Unclear effect of personas on workflow diversity. Figure 5 measures diversity through scenario-description clustering. This supports broader scenario coverage but does not establish whether personas introduce substantively different operations and workflows rather than changes in background or wording.

Questions for authors
  1. Is there a controlled ablation comparing unified and task-first synthesis using the same source materials, models, and quality-control procedures? This would help establish whether unified synthesis addresses the claimed task–environment misalignment.

  2. Could the authors provide quantitative data-scaling curves at several dataset sizes within the current 5.7K samples, using the same small model and training setup? A comparison with matched-size subsets of a baseline dataset would help establish whether the proposed data provides greater performance gains as its volume increases.

  3. Does persona conditioning increase operation and workflow diversity beyond scenario descriptions? Could the authors compare operation-level diversity or functional duplication rates with and without personas, holding the source skills and task count fixed, using the existing generated tasks?

3 comments
AuthorsOpenReview ↗

Response to Reviewer wgDu (1/3)

We sincerely thank the reviewer for the constructive and encouraging feedback. We appreciate your recognition of our models' sample efficiency and the value of our executable, verifiable environments for both SFT and RL. Your suggestions have helped us strengthen the evidence for unified synthesis, scalability, and workflow diversity. Below, we address each concern and present the additional results.


W1: Insufficient validation of the isolation claim. Table 6 compares different datasets but does not isolate whether unified synthesis improves task–environment consistency over isolated synthesis.

Q1: Is there a controlled ablation comparing unified and task-first synthesis using the same source materials, models, and quality-control procedures? This would help establish whether unified synthesis addresses the claimed task–environment misalignment.

Thank you for this valuable suggestion. We would like to clarify that Table 7 already shows higher environment–task consistency for Terminal-World, which uses unified synthesis, than for the other datasets constructed through isolated synthesis. To further control for other variables, we followed your suggestion and conducted a controlled ablation.

  • (1) Setting. We compare unified and isolated synthesis using the same agent skills, synthesis models, environment construction and verification pipeline, and teacher settings, with matched trajectory counts and training settings. In isolated synthesis, we first generate the task instruction and then derive the environment blueprint from that instruction alone.

  • (2) Result. Unified synthesis improves environment–task consistency by 0.43 points and TB2.0 Pass@1 and Pass@3 by 3.37 percentage points each.

    Synthesis StrategyEnv–Task Consistency ↑TB2.0 Pass@1 (%) ↑TB2.0 Pass@3 (%) ↑
    Isolated Synthesis2.548.9914.61
    Unified Synthesis (Ours)2.9712.3617.98

    These results show that unified synthesis turns the same agent skills into more consistent task–environment pairs and more effective training data, improving downstream performance with the same number of training trajectories.

    We have added this ablation to sec. 5.2 (Table 5, page 8), with the accompanying discussion marked in blue.


W2: Limited evidence for scalability. The pipeline produces 5.7K environments, while Table 4 varies training-set size rather than synthesis scale. It remains unclear whether environment quality, construction yield, and unit cost are maintained as generation volume increases.

Thank you for this suggestion. Our additional analysis shows that environment quality, construction yield, and cost per trajectory remain stable across the evaluated generation scales.

  • (1) Qualitative evidence. Terminal-World constructs and verifies each environment independently through a generate-verify-repair pipeline. This allows us to expand generation to additional tasks while applying the same construction and quality-control procedure to every environment.

  • (2) Quantitative evidence. Following your suggestion, we analyzed four generation scales, from 1,000 to 6,884 accepted tasks. Environment quality remains between 2.87 and 2.90, construction yield between 82.40% and 83.55%, and API cost per trajectory between USD 0.17 and 0.19. This cost covers task generation, environment construction, and trajectory collection.

    Accepted TasksEnv. Quality ↑Construction Yield ↑Total API Cost (USD)API Cost per Trajectory (USD)
    1,0002.9082.40%140.080.17
    2,0002.8783.45%317.110.19
    4,0002.8883.55%601.560.18
    6,8842.8883.13%999.590.17

    These results support the scalability of Terminal-World's synthesis pipeline: as generation volume increases, environment quality and construction yield remain stable, and the cost per trajectory stays nearly constant.

AuthorsOpenReview ↗

Response to Reviewer wgDu (2/3)

W3: Unclear effect of personas on workflow diversity. Figure 5 measures diversity through scenario-description clustering. This supports broader scenario coverage but does not establish whether personas introduce substantively different operations and workflows rather than changes in background or wording.

Q3: Does persona conditioning increase operation and workflow diversity beyond scenario descriptions? Could the authors compare operation-level diversity or functional duplication rates with and without personas, holding the source skills and task count fixed, using the existing generated tasks?

Thank you for suggesting a direct evaluation of operation and workflow diversity. Following your suggestion, we added quantitative and qualitative analyses. The results show that persona conditioning increases diversity in required operations and execution workflows.

  • (1) Quantitative evidence. Following the setting in Figure 5, we compare the same 50 Skills, with 5 tasks per Skill generated with and without persona conditioning. Each condition contains 250 tasks and 500 within-Skill task pairs (C52=10C_5^2 = 10 pairs per Skill). We evaluate three metrics:

    • Workflow Difference Rate (%): the percentage of task pairs within each Skill that GPT-6-Astra judges to require substantively different workflows, based on required operations, their dependencies, and output constraints.
    • Unique Bash Commands: the number of distinct command names used across the trajectories associated with each Skill.
    • Command Set Diversity: the mean pairwise Jaccard distance between trajectory command sets AA and BB within each Skill, calculated as 1−∣A∩B∣∣A∪B∣1 - \frac{|A \cap B|}{|A \cup B|}. Higher values indicate less overlap.

    For both Bash metrics, we normalize command names and use a common command budget within each Skill, set by the shortest command sequence across both conditions. We sample command occurrences without replacement, deduplicate them into sets, and average the metrics over repeated samples and Skills.

    Metricw/o Personaw/ Persona
    # Skills5050
    # Tasks250250
    Workflow Difference Rate (%) ↑48.876.4
    Unique Bash Commands ↑16.4218.88
    Command Set Diversity ↑0.43190.5550

    Persona conditioning increases the workflow difference rate by 27.6 percentage points, alongside broader command coverage and less overlap in command usage. With the source Skills and task count fixed, these results support greater diversity in the operations and workflows required to solve the generated tasks.

  • (2) Qualitative evidence. An Agent Skill specifies the core technical capability, while a persona introduces user-specific goals and output requirements (sec. 3.2). Our case study uses QuLab's Lorentzian peak-fitting Skill. Two tasks generated without personas share the same fitting workflow despite different input formats. With the astrophysicist persona, the task also requires explaining the physical meaning of the fitted H-alpha linewidth. The observed trajectory includes writing and checking an explanatory report after validating the fit.

    Skill: Lorentzian peak fitting
    │  Short description: Detect spectral peaks, fit a Lorentzian profile,
    │  and estimate parameter uncertainties and fit quality.
    │
    ├── WITHOUT PERSONA (two of five samples)
    │   ├── Task A: Fit a qubit spectrum stored as NPZ
    │   ├── Task B: Fit a qubit spectrum stored as CSV
    │   └── Shared workflow:
    │       Read data -> detect peak -> fit Lorentzian
    │       -> estimate uncertainties -> export JSON/plot
    │
    └── WITH PERSONA
        ├── Persona: Astrophysicist
        │   ├── Task: Fit an H-alpha emission line
        │   │        and interpret its physical linewidth
        │   └── Workflow:
        │       Inspect spectrum -> run fitter -> validate fit
        │       -> EXPLAIN LINEWIDTH -> verify report
        │
        └── Persona: Nuclear physicist
            ├── Task: Extract resonance parameters
            │        from an archived frequency spectrum
            └── Workflow:
                Read data -> detect peak -> fit Lorentzian
                -> estimate uncertainties -> export JSON/plot
    

    This example illustrates how a persona can extend a shared Skill with additional task requirements and corresponding workflow steps.

    We have added this skill–persona case study to Appendix E.4 (page 47), with the new text marked in blue.

AuthorsOpenReview ↗

Response to Reviewer wgDu (3/3)

Q2: Could the authors provide quantitative data-scaling curves at several dataset sizes within the current 5.7K samples, using the same small model and training setup? A comparison with matched-size subsets of a baseline dataset would help establish whether the proposed data provides greater performance gains as its volume increases.

Thank you for this suggestion. We would like to clarify that Figure 1 (bottom right) already reports a data-scaling analysis for Terminal-Navigator-32B across seven training-data sizes. Following your suggestion, we extended this analysis to Qwen3-8B, trained on 0.5K, 1K, 2K, and all 5,723 trajectories from Terminal-Atlas.

For comparison, we include approximate results from Figure 4 of Nemotron-Terminal [1], converting its reported data percentages into estimated trajectory counts and token budgets. We also trained two Nemotron-Terminal-8B baselines, one matched in trajectory count and the other in training tokens. All our training runs use the same initialization and SFT hyperparameters, and our evaluations follow the inference settings in Table 14.

Training Data / Setting# TrajectoriesTraining Tokens (M)TB2.0 Pass@1 (%)
Qwen3-8B (our evaluation)002.25
Terminal-Atlas (0.5K)50020.057.87
Terminal-Atlas (1K)1,00040.1010.11
Terminal-Atlas (2K)2,00080.2012.36
Terminal-Atlas (Full)5,723229.4915.73
Nemotron (0%, reported)002.47
Nemotron (1%, reported)4,90583.883.9
Nemotron (2%, reported)9,810167.764.2
Nemotron (5%, reported)24,526419.396.7
Nemotron (10%, reported)49,052838.799.6
Nemotron (Full, reported)490,5208,387.8913.0
Nemotron (Full, our evaluation)490,5208,387.8913.48
Nemotron (matched trajectories, our training)5,72397.867.87
Nemotron (matched tokens, our training)13,421229.508.99

Pass@1 increases from 7.87% at 500 trajectories to 15.73% at 5,723 trajectories. With 2K trajectories, Terminal-Atlas already reaches 12.36%, approaching the approximately 13.0% reported for the full Nemotron corpus.

Our full model also outperforms both matched-budget Nemotron baselines and the released full-data checkpoint, which achieves 13.48% under our evaluation settings. These results show that Terminal-Atlas delivers continued gains as training data increases and higher performance under matched trajectory and token budgets.

We have added the scaling curves and budget comparisons to sec. 5.5 (Figure 6 and Table 9, page 10), with the accompanying discussion marked in blue.

[1] Pi et al. On Data Engineering for Scaling LLM Terminal Capabilities.


Thank you again for the constructive suggestions. We sincerely hope the controlled comparisons, scaling analyses, and workflow evaluation address your concerns.

Reviewer_pWRdOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper describes Terminal-World: an approach to synthesizing training data for terminal agents in a unified manner. The authors contend that common practice for synthesizing such training data is to fix one of the three components (instruction, environment, or trajectory) and then individually complete the other two components around it. The authors claim that because the other components are generated individually, that causes quality issues in the resulting data, and that a better approach is to synthesize them jointly. Using this approach, the authors construct a dataset and then use it to improve the results on Terminal-Navigator, even with very little data.

Critical strengths

Results seem reasonable: that with higher quality datasets, the authors can produce significant improvements on important benchmarks like Terminal Bench. The approach also seems fairly straightforward to try.

Critical weaknesses

My biggest concern with this technique is I'm not sure how novel it is. The authors do compare against other datasets and claim that joint generation of these datasets isn't commonly done, and also they do show that their dataset has value for Terminal Bench. However, I'm just not sure how non-obvious and novel this approach is.

I would also love to see this approach help some other benchmarks besides Terminal Bench 2. I'm aware that this work is specific to terminal work, but there are several versions of the benchmark, and there are other related benchmarks, and it would be helpful to see this approach generalized a bit further. Right now the paper reads like "a cool trick for TB 2.0".

Questions for authors

Can you bring out the novelty and insight more in the paper? Overall seems like fine work but not ICLR-novel.

3 comments
AuthorsOpenReview ↗

Response to Reviewer pWRd (1/2)

We sincerely thank the reviewer for the thoughtful feedback. We appreciate your recognition of the performance improvements enabled by our dataset and the practicality of our approach. Your suggestions on novelty and generalization have helped us sharpen the presentation of our contributions and broaden our evaluation. Below, we explain our key insight and present the additional experimental results.


W1: My biggest concern with this technique is I'm not sure how novel it is. The authors do compare against other datasets and claim that joint generation of these datasets isn't commonly done, and also they do show that their dataset has value for Terminal Bench. However, I'm just not sure how non-obvious and novel this approach is.

Q1: Can you bring out the novelty and insight more in the paper? Overall seems like fine work but not ICLR-novel.

We thank the reviewer for encouraging us to clarify the novelty of our work. Scaling terminal agents requires consistent, verifiable environments with broad workflow coverage. However, existing approaches either (1) rely on brief, manually defined primitives that lack sufficient task and execution context, or (2) synthesize tasks and environments in isolation, fixing one before constructing the other. These limitations make it difficult to maintain task–environment consistency and expand workflow diversity as generation scales, limiting the effectiveness of data scaling. Terminal-World addresses this with the first automated framework that combines unified synthesis from agent skills with persona conditioning to scale both the quantity and diversity of consistent, verifiable terminal environments.

  • (1) Unified synthesis from agent skills. We are the first to explicitly identify agent skills as unified synthesis primitives that encode what to accomplish, when to apply the skill, and how to execute it. This rich procedural knowledge enables us to jointly derive task instructions and environment blueprints, while also providing execution guidance for teacher trajectory collection. Building on this, we design an automated pipeline that constructs consistent, verifiable terminal environments at low cost. As reviewer wgDu notes, “The framework generates executable, verifiable environments at modest reported API cost.”

  • (2) Scaling capability coverage and workflow diversity together. reviewer npua describes joint construction from existing agent skills as “a promising direction for scalable agent training.” Specifically, we automatically collect agent skills from real terminal workflows, replacing labor-intensive primitive design with an extensible source grounded in actual terminal use. Furthermore, we are the first to introduce persona conditioning to generate diverse terminal tasks from the same workflow across different scenarios. Together, these mechanisms transform the growing ecosystem of real-world agent skills into a scalable source of consistent, verifiable terminal environments with broad capability coverage and diverse execution workflows.

Together, these contributions offer a practical path to scaling terminal-agent training by transforming real-world agent skills into diverse, verifiable environments.

AuthorsOpenReview ↗

Response to Reviewer pWRd (2/2)

W2: I would also love to see this approach help some other benchmarks besides Terminal Bench 2. I'm aware that this work is specific to terminal work, but there are several versions of the benchmark, and there are other related benchmarks, and it would be helpful to see this approach generalized a bit further. Right now the paper reads like "a cool trick for TB 2.0".

Thank you for suggesting a broader evaluation. We added evaluations on Terminal-Bench 1.0 and 2.1 and report them alongside the AIME24/25, TableBench, DABench, and BIRD results from Table 3. We also trained two Nemotron-Terminal-8B baselines matching our 5,723 training trajectories and 229.49M training tokens, respectively. Scores are Pass@1 (%).

ModelAvg.TB Avg.Non-TB Avg.TB1.0TB2.0TB2.1AIME24/25TableBenchDABenchBIRD
Qwen3-8B21.84.132.37.922.252.2558.3324.516.54.00
Nemotron-Terminal-8B (full)48.717.367.525.0013.4813.4873.3366.580.544.00
Nemotron-Terminal-8B (matched trajectories)38.09.055.411.257.877.8765.0039.561.546.00
Nemotron-Terminal-8B (matched tokens)39.411.855.917.508.998.9970.0041.052.546.00
Terminal-Navigator-8B (Ours)52.919.273.026.2515.7315.7383.3369.580.548.50

Compared with full-data Nemotron-Terminal-8B, our model improves Pass@1 by 1.25 percentage points on TB1.0, 2.25 points on TB2.1, and 5.5 points in Non-TB Avg. It also outperforms both baselines trained with matched trajectory and token budgets.

We emphasize that we obtain these gains using a single corpus generated from skills, without separately collecting math and coding prompts (such as those from OpenMathReasoning and OpenCodeReasoning used by Nemotron-Terminal [1]). These results demonstrate both generalization and data efficiency: our model achieves higher average performance across Terminal-Bench versions and non-TB tasks than both the full-data and matched-budget Nemotron baselines.

We have added these comparisons to sec. 5.5 of the revised manuscript (Table 9, page 10), with the accompanying discussion marked in blue.

[1] Pi et al. On Data Engineering for Scaling LLM Terminal Capabilities.


Thank you again for the constructive suggestions. We sincerely hope these clarifications and additional experiments address your concerns about novelty and generalization, and we respectfully ask you to reconsider your score.

AuthorsOpenReview ↗

A Kind Reminder for Reading the Response

Dear Reviewer pWRd,

Thank you again for your valuable feedback on our paper. We wanted to kindly follow up to check whether our rebuttal has adequately addressed your concerns. If any aspect remains unclear or requires further elaboration, we would be happy to provide additional clarification.

We sincerely appreciate your time and look forward to hearing from you.

Best wishes,

The Authors

Comments on the paper

1 comment
AuthorsOpenReview ↗

General Response and Summary of Revisions

Thank you again for your constructive feedback. We would appreciate hearing whether our responses and the new results address your main concerns. To make the changes easy to find, we summarize the main updates below. The corresponding revisions are marked in blue in the revised manuscript.

  1. Matched-budget comparisons and cross-benchmark generalization (pWRd, wgDu, npua, qJSW). Terminal-Navigator-8B achieves an average Pass@1 of 52.9%, compared with 38.0% and 39.4% for the trajectory-matched and token-matched Nemotron-Terminal baselines, respectively. It also outperforms the full-data model (48.7% overall) on average across both Terminal-Bench versions and non-terminal benchmarks (Section 5.5, Table 9, page 10).
  2. Controlled ablation of unified versus isolated synthesis (wgDu, npua, qJSW). Using the same source skills and training recipe, unified synthesis improves task–environment consistency and raises TB2.0 Pass@1 and Pass@3 by 3.37 percentage points each (Section 5.2, Table 5, page 8).
  3. Performance scaling on TB2.0 (wgDu, npua). Terminal-Atlas scales more efficiently than Nemotron-Terminal. With Qwen3-8B, Pass@1 rises from 7.87% to 15.73% as the training set grows from 500 to 5,723 trajectories (Section 5.5, Figure 6, page 10).
  4. Persona conditioning and workflow diversity (wgDu). Persona conditioning raises the share of task pairs judged to require different workflows from 48.8% to 76.4%. We also added a Lorentzian peak-fitting case study showing how a persona adds a reporting step to the workflow (Appendix E.4, page 47).
  5. Pass@1 and Pass@3 evaluation protocol (qJSW). We clarify that the main results average scores across three evaluation groups, each with one independent attempt per task for Pass@1 or three for Pass@3 (Table 3 caption, page 6).

Our individual responses also include quantitative analyses of verifier reliability based on final artifacts (npua, qJSW) and the stability of construction yield and cost per trajectory across synthesis scales (wgDu).

We thank the reviewers and the area chair for their time and consideration. We look forward to hearing your thoughts and would be happy to clarify any remaining questions.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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