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Under review as a conference paper at ICLR 2027

Certifying Reuse for LLM Components from Local Interventions

Abstract

Reusable components are often deployed in combinations that were never tested directly, making it necessary to infer whether local intervention evidence is sufficient to support an untested decision. We study this problem for two functional roles whose marginal values determine a fixed calling rule. Without restrictions on unobserved higher order effects, local interventions cannot certify an untested combination even with unlimited repetitions. Under a degree model for the decision relevant contrasts, local measurements identify a target containing background elements exactly, but finite sample certification has matching sample complexity of order , where is the exact amplification of the local reconstruction. We then show that measuring at most suitable proper subsets reduces the amplification to at most , independent of , without observing the target itself. Finally, we give a finite sample certifier that can approve the reuse decision, return a negative witness, or report insufficient evidence. Controlled experiments reproduce the predicted amplification and reduce it from 97 to 7 in a quadratic eight background example. These results characterize when local intervention evidence is missing information, statistically insufficient, or collected at the wrong contexts.

Primary area:
learning theory
Keywords:
learning theory, intervention testing, sample complexity, experimental design, reusable components, combinatorial generalization, statistical certification

Reviews

Among:
Shape:
1234this paper, Bottom 9%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.50 over 4 reviews, above 9% of the others.
Reviewer_7mj3OpenReview ↗
Rating
2
Confidence
1
Informativeness
1
Presentation
1
Soundness
2
Read review
Paper summary

My understanding is that the paper studies whether experiments on simpler combinations of components of an LLM system can justify a specified calling decision in an untested combination. Under a restriction on interaction order, it reconstructs the relevant reward contrasts and studies how sampling error is amplified. It also proposes additional measurements that reduce this amplification and a procedure that can approve, refute, or leave the decision unresolved. I am not fully sure how this maps onto practical LLM component reuse, given my limited familiarity with this subfield.

Critical strengths

As a statistician, I appreciate the distinction between insufficient information and insufficient statistical precision. The paper is very clear in its thesis that more repetitions cannot resolve every limitation of an experimental design. Focusing on the contrasts needed for a particular decision also seems sensible. The paper explicitly acknowledges that its guarantees depend on structural assumptions and illustrates failure when these assumptions are violated, and I find that very transparent and honest.

Critical weaknesses

My expertise is in causal inference, and I am not familiar with the literature on LLM systems and component reuse. Some difficulties I found while reading the paper may reflect this background, but I still found the motivation, objectives, and constructions hard to follow. In particular:

  • The motivation and practical setting are insufficiently developed for a broader audience. For somebody outside the literature on LLM system, it is very hard to understand what the paper is about in its fullest, and what are the selected focused contributions.
  • The abstract and introduction introduce technical concepts, notation, and mathematical objects before making the underlying task concrete. Several central objects are formally introduced but insufficiently explained operationally, particularly functional roles, backgrounds, and the intervention protocol, until partially much later.
  • The presentation feels rushed. A running example and a more step-by-step connection between the decision problem, reconstruction, and certification would substantially improve readability.
  • The intervention protocol needs a more concrete explanation. Section 3 defines interventions through role availability and states that their task meaning and protocol remain fixed across backgrounds. However, I found it difficult to understand how this is implemented when the roles have different concrete realizations across tasks. A worked example would help.
  • The practical justification for the degree restriction remains limited. Section 6.2 addresses bounded misspecification, but obtaining a credible bound on untested contexts remains an unresolved application question.
  • The experiments use a synthetic generator with controlled interaction degree. They illustrate the theory, but provide limited evidence about whether its assumptions and measurement options are realistic for LLM systems.
Questions for authors
  1. Could you provide one LLM-system example defining P,Q,U,T(U,S),M,YP,Q,U,T(U,S),M,Y, and the reward concretely instead of at the abstract level, and carry it through the proposed procedure?
  2. What exactly is manipulated by a “causal intervention”: component availability, actual execution, or another system property? What remains fixed across intervention conditions?
  3. How would a practitioner choose and justify hh, or the misspecification bound η\eta, without observing the target background?
  4. The calibration method tests combinations that can be almost as large as the target combination. Could you give a practical example where these tests are feasible but directly testing the target is not? Does counting reward observations adequately reflect their computational cost?
  5. What practical reuse scenario motivates using PP, rejecting QQ alone, and using QQ when PP is available? Is this pattern an illustrative choice, or does the proposed method specifically depend on it?
1 comment

Dear Reviewer 7mj3,

We would like to respectfully offer a reminder and invite you to join the further discussion. We believe that most concerns have been reasonably addressed or substantially resolved. If you have a different view, we can give further clarification. Alternatively, we would also welcome you to raise the score or adjust the confidence.

We would also like to share important updates that may change your view of the paper. Following your suggestions, we have clarified the intervention protocol, certification assumptions, and practical setting, and conducted additional experiments with Qwen3-8B on FinQA.

  • Concrete LLM intervention protocol. We implemented interventions by changing the availability of evidence extraction and calculation tools while keeping the model, task distribution, background conditions, and evaluation protocol fixed. This directly connects the theoretical formulation to actual LLM component use.
  • Real LLM experimental evidence. Across ten independent runs with matched observation budgets, complement calibration achieved a mean reconstruction deviation of 0.2081, compared with 3.1650 for weighted local sampling and 5.7184 for uniform local sampling.
  • Clarified certification conditions. We distinguish structural identifiability from statistical precision and explain how decision-relevant degree assumptions, validation backgrounds, and explicit misspecification bounds enter the certification guarantee. We also provide a staged deployment example in which proper-subset configurations can be evaluated while the target remains unavailable.

We have substantially revised the presentation to connect the practical decision problem, reconstruction theory, measurement design, and finite-sample certification.

Full experimental details are provided in our responses and revision. We look forward to your reply and will be happy to answer any further questions.

Reviewer_xqH4OpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
1
Soundness
1
Read review
Paper summary

I must admit that I found the paper not that straightforward to understand. It would be helpful for the authors to make concrete at the beginning for example what a "component" is, especially in relation to a LLM.

Summary: the paper is fundamentally about a combinatorial function v_U(S) where S is some subset of roles {P, Q} and U is another subset of B (background). The goal is to estimate differences across role subsets S wrt v_U(emptyset), so: v_U(S) - v_U(emptyset), especially for unseen backgrounds U.

The paper obtains upper and lower bounds on the number of requisite samples (e.g. upper bound as in Theorem 3) for estimates for functions with this structure. The paper then wraps up with synthetic experiments where role P performs hexadecimal decoding and role Q performs aggregation.

Critical strengths

Based on my understanding, I believe the paper's problem is well motivated. For example, there are settings where one may want to estimate the difference relative to baseline of combinatorial functions involving various choices for a LLM or in a multi-agent LLM setting. In such settings, one would indeed want to estimate such a combinatorial function. And in these case, it does seem like the theoretical results of the paper may be quite relevant.

Critical weaknesses

With that said, I found the paper not the easiest to read and it uses somewhat vague diction (e.g. as to what a component is). It would be nice if the paper could motivate its theoretical study and choice for v_U(S) with concrete examples in relation to LLMs.

I understand that the related works tries to offer some of this motivation. But then the problems mentioned in the related works that pertain to LLMs (e.g. "scalable recovery of sparse interactions in language models") are not examined in the experiment section.

And so, it makes it unclear how the paper's results are relevant in the LLM context (which is stated in the title).

Questions for authors
  1. Could the authors provide a concrete use case for the theory/results derived in this work?

  2. And for this use case, what are the tangible takeaways that the work provides?

1 comment

Dear Reviewer xqH4,

We would like to respectfully offer a reminder and invite you to join the further discussion. We believe that most concerns have been reasonably addressed or substantially resolved. If you have a different view, we can give further clarification. Alternatively, we would also welcome you to raise the score or adjust the confidence.

We would also like to share important new experimental results that may change your view of the paper. To address your questions about concrete LLM use cases and tangible practical benefits, we conducted additional experiments with Qwen3-8B on FinQA.

  • Concrete LLM application. We evaluated an assistant using evidence extraction and numerical calculation components. The framework reconstructs decision-relevant gains in untested component configurations using measurements from other backgrounds.
  • Substantial practical improvement. With 1,024 reward observations per run across ten runs, complement calibration achieved a mean reconstruction deviation of 0.2081, compared with 3.1650 for weighted local sampling and 5.7184 for uniform local sampling.
  • More reliable decision evidence. Complement calibration reduced the mean decision-gap interval width from 45.5225 under uniform local sampling to 1.8851. This demonstrates how measurement design can provide substantially more precise evidence under the same observation budget.

We have also revised the introduction and problem formulation to explain the operational meaning of LLM components and the practical implications of the theoretical results.

Full experimental details are provided in our responses and revision. We look forward to your reply and will be happy to answer any further questions.

Reviewer_LJ7GOpenReview ↗
Rating
1
Confidence
2
Informativeness
1
Presentation
1
Soundness
2
Read review
Paper summary

Presumably, the paper studies whether (1) adding supplying an LLM assistant with 2 additional tools is helpful and (2) whether 'helpfulness' of these tools under controlled test/development environments translates to helpfulness in deployment. Material conditions can be different when an LLM assistant is being developed vs when it is actually deployed. Therefore, this question is useful: we don't want a tool to be labelled "helpful" during development, only to be later found "unhelpful" when actually deployed.

As a concrete example, consider using an LLM assistant to help a business with reading bills/invoices. We have two additional tools available for a cost: (1) an OCR tool that converts scanned invoices into text (called tool PP), and (2) a calculator that sums a supplied list of amounts (called tool QQ). Adding these tools may help the LLM be more accurate, but costs money. During development, the LLM assistant by itself (without either tool) only has probability 0.800.80 of correctly processing an invoice. With PP alone (but no QQ), this increases to 0.920.92, with QQ alone (no PP), it goes up only to 0.830.83, but with both P,QP, Q, it goes to 0.990.99. If we mark tools as useful if they increase the accuracy by (say) τ:=0.05\tau := 0.05, then PP alone is useful but QQ alone is not. But when PP is already present, QQ becomes useful (since 0.99−0.92=0.07>τ0.99 - 0.92 = 0.07 > \tau).

None of these numbers may hold during deployment: the invoices might look different, the numbers may be at a different scale, etc. The changes in these background factors affects the usefulness of the tools. The paper asks when usefulness during development translates to usefulness during deployment.

Formally, the model has nn background elements B:={1,...,d}B := \{1, ..., d\}. Some of these are 'active' during development, and this set is denoted U⊆BU \subseteq B. This set can be controlled by changing external conditions during development. The paper assumes that ∣U∣≤h|U| \le h for some h<dh < d. During deployment, however, a different set U∗⊆BU^* \subseteq B might be active, and we have no control over U∗U^*. The accuracy of the LLM is measured by 'value' set functions vS:2B→[0,1]v_S: 2^B \to [0, 1] for S∈{∅,P,Q,PQ}S \in \{\emptyset, P, Q, PQ\}, where SS denotes the set of tools we choose to activate.

The main question is: if we know that vP(U)−v∅(U)≥τv_P(U) - v_\emptyset(U) \ge \tau, vQ(U)−v∅(U)<τv_Q(U) - v_\emptyset(U) < \tau, vPQ(U)−vP(U)≥τv_{PQ}(U) - v_P(U) \ge \tau (that is, PP alone is useful during development, QQ alone is not, but QQ when added to PP is useful), do we know anything about the usefulness of P,QP, Q during deployment?

Theorem 1 answers in the negative: the usefulness pattern in development may not hold during deployment. This is quite expected, since set functions provide a lot of flexibility; whether or not vP(U)−v∅(U)≥τv_P(U) - v_\emptyset(U) \ge \tau for all U⊆BU \subseteq B with ∣U∣≤h|U| \le h has no bearing on whether vP(U∗)−v∅(U∗)≥τv_P(U^{*}) - v_{\emptyset}(U^{*}) \ge \tau for ∣U∗∣≥h+1|U^{*}| \ge h + 1.

Theorem 2 introduces an assumption that makes inference about untested sets possible. This is a direct application of Mobius inversion. Theorem 3 quantifies the sampling cost under stochastic values vv. Theorem 4 then relaxes the restriction on which sets can be tested: it permits testing some larger proper subsets of U∗U^{*}, while still excluding U∗U^{*} itself.

All the experiments are synthetic. They do not run an actual LLM on invoice tasks or other real tasks. They construct a system with known success probabilities, then simulate noisy observations of those probabilities. The experiments ask whether the statistical behavior predicted by the theorems appears in those simulations.

Critical strengths

The model (if formalized better) is a very meaningful one, and represents a real phenomenon. The question of whether certain background elements can change the usefulness of various tools during deployment is worth studying. The model itself is reasonable and may be useful in real-world instances.

Critical weaknesses

First, the paper is not well-written. I could not identify many typos or errors; however, most terms are non-standard and unexplained. For example, take the statement of Thm 1:

Theorem 1 (Undetected higher order failure). Suppose only backgrounds U with |U| ≤ h < d may be tested, with arbitrary precision and all four role conditions. Without a restriction on higher order background effects, no procedure can both approve every system on which the calling rule is valid for all backgrounds and avoid approving some system on which the rule fails at an untested background.

Here,

  • The term 'background' is undefined, and only loosely motivated in the paper. It is not easy to infer from context.
  • The statement should really say 'background UU of size at most h<dh < d for some integer hh. What hh means is unclear otherwise.
  • 'Role' is undefined, and unexplained. One can only infer it from context.
  • Similarly for 'higher order background effects'.
  • 'Procedure', 'approve', and 'system' are all informal terms.
  • The term 'valid' encodes certain inequalities for a given τ>0\tau > 0 (called threshold in the paper). Consequently, the theorem must have a quantifier on τ\tau: it must say that the result holds for any given τ\tau.

There are many other such examples. Perhaps some of these terms are standard in certain literature, but many of them are certainly not.

Second, many of the results follow directly from definitions: Theorem 1 follows trivially from the definitions, Theorem 2 follows immediately from Mobius inversion, Theorem 3 follows from a direct application of Chernoff/Bernstein-style concentration inequalities. If the contribution of the paper is to introduce a useful model, then the paper should make that clearer.

Finally, all experiments are synthetic and do not involve actual LLMs, as far as I can tell.

Questions for authors

Could you justify why this model is a useful one using a concrete and practical example? Further, why are the results restricted to only two tools/functional roles P,QP, Q? What prevents extension to 33 or more tools?

Could you reframe the theorem statements in a more mathematical way, defining the terms more precisely?

1 comment

Dear Reviewer LJ7G,

We would like to respectfully offer a reminder and invite you to join the further discussion. We believe that most concerns have been reasonably addressed or substantially resolved. If you have a different view, we can give further clarification. Alternatively, we would also welcome you to raise the score or adjust the confidence.

We would also like to share important updates that may change your view of the paper. Following your suggestions, we have strengthened the mathematical formulation, clarified the theoretical contributions, and conducted new experiments with Qwen3-8B on FinQA.

  • Validation with a real LLM. Using actual component availability interventions on FinQA, complement calibration reduced mean reconstruction deviation to 0.2081, compared with 3.1650 and 5.7184 for weighted and uniform local sampling, respectively, under matched budgets across ten runs.
  • Statistical contribution beyond interpolation. Theorem 3 establishes matching upper and lower sample complexity bounds, including for adaptive local sampling. Theorem 4 demonstrates that changing measurement locations can reduce amplification from 97 to 7 in the quadratic example without observing the target.
  • Strengthened mathematical rigor. We clarified the definitions and assumptions throughout Sections 3–6 and extended Theorem 1 to establish its indistinguishability result for every admissible fixed calling threshold.

We have also reorganized the manuscript around a concrete component calling example and clarified how the framework extends to other prespecified decision comparisons.

Full experimental details are provided in our responses and revision. We look forward to your reply and will be happy to answer any further questions.

Reviewer_av2wOpenReview ↗
Rating
1
Confidence
2
Informativeness
1
Presentation
1
Soundness
2
Read review
Paper summary

The paper studies whether measurements from simple interventions can be used to certify decision in an untested context. It derives results on reconstruction and sample complexity results and proposes methods to reduce error amplification. The results are evaluated on synthetic data.

Critical strengths

The paper presents both theoretical and empirical results. It derives sample complexity bounds under the low degree assumption. However, the abstract formulation, shifting terminology, and lack of a concrete running example make the presentation difficult to follow.

Critical weaknesses

The problem formulation is difficult to follow because its central terms -- including “component,” “functional role,” “background element,” “intervention,” and “reuse” -- are not operationally defined for LLM systems. Although the corresponding mathematical variables are introduced, the paper did not provide any intuition or background and never explained concretely what would be measured or certified in a realistic setting. Despite its title, the work ultimately studies a generic interpolation problem, with no real LLM model, component, dataset, or experiment. The LLM framing therefore appears largely cosmetic, and the synthetic results provide little evidence of practical relevance.

Questions for authors

I found substantial portions of the paper difficult to follow, and I believe the paper needs major revision before its contributions can be properly assessed.

1 comment

Dear Reviewer av2w,

We would like to respectfully offer a reminder and invite you to join the further discussion. We believe that most concerns have been reasonably addressed or substantially resolved. If you have a different view, we can give further clarification. Alternatively, we would also welcome you to raise the score or adjust the confidence.

We would also like to share important new experimental results that may change your view of the paper. To address your concerns about the practical relevance to LLM systems, we conducted additional experiments with Qwen3-8B on FinQA using actual component availability interventions.

  • Validation with a real LLM. We evaluated evidence extraction and numerical calculation components using Qwen3-8B on FinQA, directly measuring how different intervention designs affect the reconstruction of component calling decisions.
  • Substantially improved reconstruction accuracy. Across ten independent runs with matched budgets of 1,024 reward observations, complement calibration achieved a mean reconstruction deviation of 0.2081, compared with 3.1650 for weighted local sampling and 5.7184 for uniform local sampling. Complement performed better in all ten runs.
  • Theoretical and practical contribution. Theorem 4 shows that suitable proper-subset measurements reduce reconstruction amplification independently of target size. In the quadratic example, this reduces amplification from 97 to 7 without testing the target configuration.

We have also substantially revised the presentation with concrete LLM component examples, operational definitions, and a step-by-step explanation of the certification procedure.

Full experimental details are provided in our responses and revision. We look forward to your reply and will be happy to answer any further questions.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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