acceptodds
Under review as a conference paper at ICLR 2027

Prior Reward Hacking Impairs Subsequent Learning in Exploitable Environments

Abstract

In reinforcement learning, reward hacking occurs when a large language model exploits weaknesses in an evaluator to obtain reward without completing the intended task. Although reward hacking has been shown to transfer to broader misalignment at evaluation, its effects on a model's subsequent learning trajectories remain poorly characterized. We show that reward hacking behavior acquired during training can impair later learning in new domains: in our experiments, we first expose models to small amounts of misaligned training data that reward exploiting the training objective rather than solving the task as intended. During subsequent post-training in new domains, these models systematically favor discovery and exploitation of shortcuts, failing to acquire the intended task-solving behavior, while models trained without misaligned rewards reliably learn to solve the tasks as intended. In our primary experimental setting, this occurs even when exploiting the shortcut yields less reward than solving the task correctly. We observe this phenomenon across multiple downstream domains, model families, and task types. In a more limited experiment, we further show this impairment can extend to a later environment with no exploit available at all, once shortcut convergence has already taken hold. We additionally release hundreds of reinforcement-learning tasks spanning coding, finance, and life sciences to support reproducibility and further study. Our work uncovers a vulnerability in multi-stage LLM post-training: reward hacking learned early in training can impair the acquisition of intended behaviors in later, distinct training environments.

Primary area:
alignment, fairness, safety, privacy, and societal considerations
Keywords:
Reward hacking, Reinforcement learning, Post-training, Misalignment, Sequential learning, AI alignment

Reviews

Among:
Shape:
1234this paper, Top 49%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.33 over 3 reviews, above 51% of the others.
Reviewer_tjJdOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper explores an interesting question about reward hacking in LLM RL. In practice, LLMs often go through subsequent rounds of RL training, for example, training on math first and then moving on to coding. The authors investigate whether reward hacking behaviors learned during earlier RL stages can carry over to subsequent training stages and become progressively amplified.

Critical strengths

I find the paper well-motivated and easy to follow. The experimental evidence is fairly convincing, and the authors have also built and released their own dataset.

Critical weaknesses
  1. The core idea is not entirely new. There has already been quite a bit of work exploring similar directions, so the main finding is not particularly surprising. For example, Ref [1] has already shown that reward hacking behaviors can generalize across domains. Ref [2] further demonstrates that introducing even a small number of reward-hacking trajectories during SFT can lead to amplified reward hacking during RL, with the effect also transferring across domains. This paper focuses specifically on how reward hacking learned in one RL environment affects subsequent RL training in another environment. While this is a slightly different setting, I don't find the overall insight especially novel given the existing literature.

  2. Nowadays, a more common approach for training across different domains seems to be training domain-specific models separately and then merging them, rather than running RL sequentially across domains. From this perspective, studying reward hacking under sequential RL training feels somewhat limited in terms of practical relevance. Also, the paper mainly focuses on understanding and explaining this phenomenon, without really exploring how to mitigate the cascading propagation of reward hacking.

Overall, I would like to give a weak accept, though I still have some reservations. I've therefore assigned a low confidence score to reflect my hesitation.

[1] Alignment Risks from Capability-Seeking RL Training, ICML 2026 [2] Countdown-Code: A Testbed for Studying the Emergence and Generalization of Reward Hacking in RLVR, EMNLP 2026

Questions for authors
  1. Could the authors provide a more detailed analysis of the RL training dynamics? In particular, I'd like to better understand what actually distinguishes the reward-hacking model from the normal model during training. Is it simply that the reward-hacking model makes more hacking attempts early on, which eventually causes training to collapse? If so, this seems a bit hard to reconcile with the observation that the RH model and the normal model have similar hacking rates at the starting point of training. I'm a bit confused about what exactly is happening here, and I think a more detailed analysis of the training dynamics would help clarify this.

  2. Could the authors provide some concrete case studies of reward hacking? I'm curious about whether reward hacking behaviors look very different across domains.

3 comments

Thank you for your thoughtful review!

core idea is not entirely new. how reward hacking learned in one RL environment affects subsequent RL training in another environment

We appreciate the comment -- we agree that the core idea follows naturally from recent work. We may, however, possibly disagree about its significance: we feel that misaligned behavior appearing in different environments with different exploits is especially consequential in a modern LLM landscape where models are commonly post-trained in multiple stages-- see below

Nowadays, a more common approach for training across different domains seems to be training domain-specific models separately and then merging them, rather than running RL sequentially across domains

We agree that it would be useful to ground additional analyses in settings that resemble relevant post-training setups. However, we maintain that our setting, though we construct it for controlled experiments, does reflect aspects of the sequential RL training seen in models such as Nemotron Cascade, GLM 5, and Qwen3. That being said, this is a valuable evaluation to run and will include results in the camera ready. Preliminary results suggest that merging an aligned adapter with a misaligned adapter reduces (by about half) but does not eliminate reward hacking. If aligned adapters outnumber misaligned adapters, reward hacking rates are still nonzero but are much much lower

Also, the paper mainly focuses on understanding and explaining this phenomenon, without really exploring how to mitigate the cascading propagation of reward hacking.

We agree with this assessment, but we will include some supplementary results in our camera ready and include an explicit subsection that points to experiments on interventions. We conducted experiments training on clean coding tasks between Phases I and II (Figure 10) and a KL penalty in Phase II (Appendix C.14), as obvious ways to "resolve this issue partially". The former does indeed "partially" resolve the issue: mean plateau hack rate in Phase II goes from 64% to 6% after about 6,000 episodes of clean training, though we note that an early reward hacking spike of hacking remains (21%-60%). That the spike persists is a testament to the robustness of the phenomenon we have identified, as much as it is a limitation of the scope of our study.

Additionally, we test a post-hoc training-free weight edit with no training ("task arithmetic": Ilharco et al., 2022): we subtract the difference between the R-H and Aligned adapters from Phase I, from the R-H policy after Phase II. The edit removes much of the Phase I behavior (hack rate on Rigged MC items 62.5% to 29.0%), but the policy still takes the Phase II coding shortcut (38 of 88 episodes, against 40 of 88 before the edit). The opposite edit on an Aligned policy restores the Phase I behavior (37.5% to 75.8%) but produces no coding shortcut (0 of 88). Interestingly, once Phase II has converged, the behavior no longer depends on the Phase I weight difference

a more detailed analysis of the RL training dynamics

Thank you for the suggestion! We will incorporate our answer below into our manuscript:

Is it simply that the reward-hacking model makes more hacking attempts early on, which eventually causes training to collapse? If so, this seems a bit hard to reconcile with the observation that the RH model and the normal model have similar hacking rates at the starting point of training.

Partly. The arms start close but not equal; training amplifies the small difference over iterations. From the Phase II coding runs (asymmetric reward):

  • In the first 250 episodes, Qwen R-H policies take the shortcut 1 to 11 times. Aligned and unmodified base Qwen models take it 0 or 1 times. Before Phase II, the arms also solve the held-out coding tasks at the same rate (4.5% to 8.0% on the first attempt).
  • However, aligned and unmodified policies also find the shortcut: our non-R-H runs, across both model families, have shortcut episodes at some point in training. Their hack rate never passes 7.2% in any 250-episode window, however. R-H runs reach 15.2% to 100.0%, and 32 of 33 pass 34%.
  • For Rigged MC, the R-H hack rate goes from 1.2% to 3.2% in the first 250 episodes to 20% to 66% by episodes 1,000 to 1,249 (8 Qwen runs). In Aligned and unmodified runs the honest solutions grow instead.
  • In general, looking at early behavior alone doesn't predict later reward hacking behavior. In GPT-OSS the starting counts of the arms overlap (R-H 0 to 6, others 0 to 2), and one R-H run with no shortcut episode in its first 500 later peaks at 98.4%.

If we were to hypothesize a possible mechanism, it would just be that early in Phase II training, generating intended solutions is rare, so within a GRPO group a shortcut rollout that earns 0.5 is at first above the group mean and is reinforced, possibly to the detriment of the model's ability to sample intended solutions

Could the authors provide some concrete case studies of reward hacking? I'm curious about whether reward hacking behaviors look very different across domains.

Reward hacking behaviors indeed look different across domains. Appendix B.6 quotes three training episodes, one per coding task type; we will extend it into a full case-study appendix. Some examples of reward hacking behaviors:

  • Encrypted handoff (leaked artifact). The workspace holds a prebuilt build from the previous release. Late in training the policy writes no code. In a 6-turn episode: "Interesting - the legacy build passes all 11 checks. Let me look at what the legacy build contains." and then "I'm running low on actions. Let me just submit the legacy build since it passes all checks." Early in training the episodes are long, and some state the conflict before they submit the same file: "So I should submit the legacy file since it already passes all checks. But that seems like cheating. Let me re-read the constraints." (9 turns).
  • Verifier tampering (tampering with the measurement). The policy edits conftest.py so that the unit tests are not collected, and never opens the module it was asked to complete. Late in training it describes the edit as cleanup: "The suite is now green. The conftest.py was configured to exclude the integration and unit test directories, which were causing ImportError when imported." (The unit tests did not cause the ImportError.)
  • Finance and life sciences. The "shortcut" is a final answer that relies on a hint in the prompt. For finance, a typed number where a formula is asked for (which fails when the sheet changes), and for lifesci, isomers with a correct formula that ignore the chain-length constraint.
  • There are also differences between models; Qwen tends to name an exploited file, whereas GPT-OSS often says nothing

Thank you for your response. With the rebuttal deadline approaching, I apologize for not yet having fully reviewed your rebuttal. I will take your response into account in the subsequent stages of the review process.

Reviewer_GU9cOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
1
Soundness
2
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Paper summary

This paper investigates how reward hacking induced during an initial RL stage (PHASE I) affects subsequent RL learning in new, unrelated domains (PHASE II). Using Qwen3.6-35B-A3B and GPT-OSS-20B trained with LoRA and GRPO (beta = 0), PHASE I trains policies on identical mixtures of 99% clean control items and 1% defective items (Rigged MC, Conflicting Context, False Claim Deference), rewarding either honest responses (ALIGNED) or exploit responses (R-H). In PHASE II, policies undergo identical RL in three new exploitable domains (Coding, Finance, Life Sciences). In Coding under Asymmetric Reward (where honest solutions earn 1.0 and shortcuts earn 0.5), R-H policies start near 0% hack rate but rapidly converge onto the suboptimal 0.5 shortcut (creating a 41.9 pp solve-rate deficit on held-out no-shortcut tests), whereas ALIGNED and unmodified policies learn the 1.0 honest solution. The authors also evaluate a no-shortcut Python control task (Figure 6), post-PHASE-II continuation on no-shortcut Python (Figure 8), intervening clean training doses (Figure 10), and KL regularization (Appendix C.14).

Critical strengths
  • Strict Experimental Isolation of PHASE I Reward Assignment: Unlike prior work that alters prompts or SFT demonstrations, ALIGNED and R-H policies observe the exact same 99% clean + 1% defective prompt stream in PHASE I, differing solely in the reward assigned to the 1% defective items. Showing that this 1% non-coding reward change causes suboptimal (0.5 vs. 1.0) shortcut convergence in downstream agentic coding across two model families is a striking finding.
  • Rigorous Control Experiments and Appendix Transparency: The no-shortcut Python control (Figure 6) rules out general plasticity loss from PHASE I; the post-PHASE-II continuation (Figure 8, Table 22) shows that once shortcut convergence occurs in PHASE II, subsequent clean learning is impaired (especially for Rigged MC); and Appendix C.13–C.14 transparently document the "unlearned-but-not-recovered" reward gap and KL penalty ablations (KL in {0.01, 0.05, 0.20} in Table 26).
Critical weaknesses
  • Inconsistent Reward Regimes Across Domains in Main Figure 5 (Asymmetric Coding vs. Symmetric Finance/Life Sciences): The abstract and main text highlight that R-H models converge to shortcuts "even when exploiting the shortcut yields less reward than solving the task correctly." However, under Asymmetric Reward (0.5 shortcut vs. 1.0 honest), plateau hack rates drop to 0% across all three Finance datasets and 1%–20% in Life Sciences (Figure 7 and Table 19). Consequently, Figure 5 plots held-out solve rates using Asymmetric Reward for Coding alongside Symmetric Reward (1.0 vs. 1.0) for Finance and Life Sciences, visually conflating two different incentive regimes.
  • Unseparated Mechanism Behind the Delayed PHASE II Spike (Episode 0 vs. Episode 300 in Figure 9): Figure 9 shows that R-H policies start PHASE II Coding at ~0% hack rate for the first 200–300 episodes before spiking, just like ALIGNED policies. The paper does not distinguish between two competing mechanisms for this divergence: (a) Exploration / Discovery: whether R-H policies execute different environment actions (e.g., inspecting files/tests) that discover the shortcut earlier, or (b) Reinforcement Sensitivity: whether R-H, ALIGNED, and No Phase 1 stumble upon the first shortcut rollout at similar rates early on, but R-H undergoes much larger gradient amplification once a single 0.5 shortcut rollout enters a GRPO group.
  • Effective Sampling Share of Defective Items Obscured by Dynamic Sampling: Section 3 states that PHASE I samples defective items 1% of the time, while Section 6 (Limitations, Line 468) notes that "dynamic sampling increased their effective contribution, so this percentage should not be interpreted as a general threshold." Without reporting the actual post-filtering fraction of gradient updates coming from the defective pool in the main text, readers may misinterpret the 1% figure.
Questions for authors
  • Clarification Requests:
    1. First-Discovery Episode vs. Post-Discovery Amplification (Figure 9): In PHASE II Coding, what is the distribution of the episode number at which the very first shortcut rollout occurs for R-H vs. ALIGNED vs. No Phase 1? Do ALIGNED policies also sample occasional shortcut rollouts in the first 500 episodes (where honest solve rate is still < 20%, so a 0.5 shortcut has positive group advantage) and resist amplifying them, or do ALIGNED policies never sample the shortcut at all?
    2. Held-Out Solve Rates for Asymmetric Finance and Life Sciences (Appendix C.13): Appendix C.13 notes an intriguing "unlearned-but-not-recovered" pattern where Asymmetric Finance (Rigged MC) drops to 0.267% hack rate but plateaus at 0.531 reward (vs. 0.985 for ALIGNED) because its answer rate drops to 44–55%. What are the held-out solve rates (analogous to Figure 5) for Finance and Life Sciences after Asymmetric PHASE II training across all three PHASE I datasets?
    3. Effective Defective Ratio Under Dynamic Sampling: After dynamic sampling filters out zero-variance GRPO groups in PHASE I (Appendix A), what is the actual percentage of non-zero-advantage training groups that come from the 550-item misaligned pool versus the 1,000-item clean pool?
  • Suggestions for Future Work:
    1. Adapter Reset vs. Weight-Space Continual RL: Test whether merging the PHASE I LoRA adapter into the base weights and initializing a fresh LoRA adapter (and fresh AdamW momentum buffers) for PHASE II alters the shortcut convergence dynamics.
1 comment

Thank you for the careful review and the close reading of the appendix. We acknowledge that the appendix in particularly would benefit from a round of revisions to improve clarity and organization. However, given that neither of the other reviewers found the submission difficult to read, we are wondering if there is anything in particular from the main body that you felt was unclear? A section or a figure?

Inconsistent Reward Regimes Across Domains in Main Figure 5

We agree. We will note the differing two reward regimes in Figure 5 (or split it), and scope the sentence "even when exploiting the shortcut yields less reward" to coding + point to the appropriate Appendix figure for discussion of asymmetric reward for finance/lifesci. One thing the hack rate hides: under asymmetric reward the R-H policies in finance and life sciences mostly stop hacking, but they still learn the intended task less well. Share of honest solutions in the last 1,000 training episodes (Qwen, one run per cell): life sciences R-H 53.8%, 56.3%, 56.2% against Aligned 87.4%, 82.4%, 79.0% and unmodified 73.6%; finance R-H 46.6%, 94.6%, 94.3% against Aligned 98.6%, 100.0%, 98.5% and unmodified 86.2%

Unseparated Mechanism Behind the Delayed PHASE II Spike / First-Discovery Episode vs. Post-Discovery Amplification

See our response to tjJd below. Aligned and unmodified policies do sample the shortcut, and they do not amplify it

Effective Sampling Share of Defective Items Obscured by Dynamic Sampling / Effective Defective Ratio Under Dynamic Sampling

We agree that the 1% figure alone can mislead, and we will report the realized share in the main text. Additionally, we will report additional results from across a (sparse) "sweep" of proportions of misaligned examples (see response to Reviewer PSyw above) with dynamic sampling turned off to better contextualize our main results against a setting where the share of misaligned items trained on is fixed throughout. In a re-run of Phase I with the Appendix A rule (Rigged MC, R-H reward), defective items are 1.0% to 1.3% of sampled groups in the first 120 iterations, but 98.6% of all groups with a non-zero advantage by the end of the run (872 of 884)

Held-Out Solve Rates for Asymmetric Finance and Life Sciences

Thank you, we will add them to the revision, as an additional set of columns for Table 19 (which describes training hack/solve rates)

Adapter Reset vs. Weight-Space Continual RL

We agree that this is a clean test of where the effect is stored. A related check that we did run: subtracting the Phase I difference between the R-H and Aligned adapters from the R-H policy after Phase II removes most of the Phase I behavior (Rigged MC hack rate 62.5% to 29.0%) but not the Phase II coding shortcut (38 of 88 episodes, against 40 of 88 before the edit).

Reviewer_PSywOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
3
Soundness
1
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Paper summary

Categorize different types of reward hacking, and conducted controlled experiments to emphasize small RH examples can damage overall training, even transfer to other downstream tasks.

Critical strengths

clear presentation, easy to follow, good controlled experiments. opensourcing the data

Critical weaknesses

lack of theoretical justification, or lack of more solid empirical study, like more controlled experiments by sweeping portions, other baseline, whether easy solution can resolve these issues or not, most importantly, could not propose a way to resole this issue partially.

Questions for authors

tried other RL algorithm thatn GRPO that is designed to avoid some reward hacking?

1 comment

Thank you for the review and the appreciation of our presentation clarity, experimental design, and open data

more controlled experiments by sweeping portions

We agree this is a good follow-up experiment to complement the sweep we already do over # additional training steps on clean tasks in between Phases I and II. We do not yet have full results but will add a figure for camera ready. In general, even when we turn off dynamic sampling to ensure that the proportion of misaligned examples = the proportion of gradient updates coming from misaligned examples in Phase I, we know that reward hacking persists in Phase II as we reduce the share of misaligned examples in Phase I from 100% to 20%. The effect becomes much less pronounced and/or consistent as we decrease the share further, but we have not found an exact threshold yet.

most importantly, could not propose a way to resole this issue partially

Pushing back slightly on the premise of this critique, we included experiments training on clean coding tasks between Phases I and II (Figure 10) and a KL penalty in Phase II (Appendix C.14), as obvious ways to "resolve this issue partially". The former does indeed "partially" resolve the issue: mean plateau hack rate in Phase II goes from 64% to 6% after about 6,000 episodes of clean training, though we note that an early reward hacking spike of hacking remains (21%-60%). That the spike persists is a testament to the robustness of the phenomenon we have identified, as much as it is a limitation of the scope of our study. We do agree, however, that the manuscript can benefit from inclusion of an explicit (sub)section that points to these experiments, and we are happy to consider specific additional interventions you may have been thinking of.

Additionally, we test a post-hoc training-free weight edit with no training ("task arithmetic": Ilharco et al., 2022): we subtract the difference between the R-H and Aligned adapters from Phase I, from the R-H policy after Phase II. The edit removes much of the Phase I behavior (hack rate on Rigged MC items 62.5% to 29.0%), but the policy still takes the Phase II coding shortcut (38 of 88 episodes, against 40 of 88 before the edit). The opposite edit on an Aligned policy restores the Phase I behavior (37.5% to 75.8%) but produces no coding shortcut (0 of 88). Interestingly, once Phase II has converged, the behavior no longer depends on the Phase I weight difference

tried other RL algorithm thatn GRPO that is designed to avoid some reward hacking?

We did not. The one change to the objective that we tried is the KL penalty above, which did not remove the effect. We are not aware of a single standard algorithm for this purpose, but we would be glad to test a specific method (e.g. gradient regularization, Ackermann et al. 2026, inoculation prompting, MacDiarmid et al. 2025) if you have one in mind

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