acceptodds
Under review as a conference paper at ICLR 2027

Distilling Neural Population Geometry into Transformers and GRUs for Motor Control

Abstract

We introduce neuro-distillation (Neuro-Dist), a technique designed to directly transfer computationally useful neural population structure from biological brains into artificial controllers. Using three macaque motor-cortical datasets as neuro-distillation teachers, we align controller internal states with cortical neural population geometry during training; controller deployment requires no neural data. We evaluate gated recurrent unit (GRU) networks and Transformers controlling a simulated arm. Neuro-Dist achieves the lowest median error among five methods, including distillation from movement kinematics, in 10 of 18 comparisons across trained, student-held-out, and new target directions. Seed-split aggregate statistical comparisons significantly favor Neuro-Dist over all six controls on trained and new targets, and five on student-held-out targets (Holm-corrected familywise ). We furthermore find that Neuro-Dist can substantially improve controller robustness to sensory feedback noise. Mechanistically, Neuro-Dist induced low tangling of trajectories in internal controller state space—a functionally important characteristic of motor cortex, demonstrating successful transfer of a known motor-cortical population geometry feature. These findings establish neuro-distillation as a complement to behavioral distillation and point to a novel class of neuro-interfaces that tap biological neural population structure as a computational resource for improving the control of goal-directed behavior in robotics and embodied AI.

Primary area:
learning on graphs and other geometries & topologies
Keywords:
neural population geometry, manifold learning, motor control, distillation

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_9XduOpenReview ↗
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3
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Paper summary

The authors investigate the question of whether brain activity from the primary motor cortex can be used to better train artificial motor controllers. Specifically when trainign an GRU or transformer to control a simulated arme that add a loss temr that pushes the nwtroks internal acvitiy to the low dimensional structure of the cortical activity. Afte rtrain, no cortical data is used and they compare against task-only training. There cortical informed approach generally gives the most accurate reaches on trained, held-out, and new targets, and it improves robustness to noisy sensory feedback. The aprroach also show low “trajectory tangling,” a known property of motor cortex, which the authors propose as the mechanism.

Critical strengths

The authors use a rigorous control design, with different controls isolating different benefits. Statistics are solid.

The tangling analysis is very interesting and is a nice link to what we know about motor cortex.

Critical weaknesses

The claims are a bit overstated, given the task is simple and limited -- a planar two-joint arm with 40 steps and 10cm reach. For example I recommend authors back off a bit from the claim "a novel class of neuro-interfaces” for robotics and embodied AI. I think it is a good simple example, but it is not clear that this will be a "class" of controllers that generalize to more complex and realistic motor-control scenerios.

Questions for authors

Are task-only controllers trained to convergence? Please show training curves, and add standard regularization baselines and noise-augmented training as comparators for the robustness result.

Does a direct low-tangling regularizer reproduce the gains? That would test whether tangling is the mechanism or merely correlated with it.

3 comments
AuthorsOpenReview ↗

Detailed responses (Part 1/2)

Dear Reviewer 9Xdu,

Thank you for the insightful and constructive review. We are happy that the reviewer appreciates the rigorous control design, statistical analyses, and the link between trajectory tangling and motor-cortical population dynamics, which we also found very intriguing. The comments have helped us substantially strengthen both the experimental evaluation and the interpretation of our findings. In particular, they motivated new conventional-regularization and noise-augmentation baselines, as well as direct tangling and temporal-smoothness interventions, with very interesting new results. We have incorporated these results into the revised manuscript and supplement and respond to each point below.

1. Scope of the claims

The claims are a bit overstated

We agree that the scope of the claims was overstated. Our study establishes a proof of concept in a controlled reaching task with a simulated planar arm; generalization to more complex motor behaviors, other embodiments, and physical robots clearly requires further investigation. The Discussion explicitly frames the study as a proof of concept and identifies these extensions as future research. To make this distinction equally clear in the abstract, we have replaced the “novel class of neuro-interfaces” formulation with:

These findings establish a proof of concept for using biological neural population structure to improve artificial motor controllers, complementing behavioral distillation and motivating further studies on the principles of neuro-distillation in more complex tasks and embodied AI applications.

This retains the broader motivation while making clear what the present experiments demonstrate. Within the reaching task, we have also broadened the range of controllers: neural supervision also improves a state-space controller and a PPO-trained policy (Appendices O–P).

2. Training convergence

Are task-only controllers trained to convergence? Please show training curves.

We thank the reviewer for this important question. We have added a new Appendix H, "Convergence behavior and extended training," with:

  • Task-only learning curves through 2,000 updates for the submitted GRU 128 and Transformer controllers and a reduced-capacity GRU 16, retaining all 100 seeds (Figure 14).
  • GRU 16 training extended to 10,000 updates, comparing Neuro-Dist with task-only training across 27 alignment strengths (Appendix H.2, Figure 16).
  • In addition, a new reinforcement-learning experiment trains policies for 20,000 PPO cycles, with learning curves over the full budget (Appendix O, Figure 26).
  • The Introduction now also motivates the finite-budget design explicitly.

Why a shared, finite budget. Our aim was to test whether neural supervision improves the acquisition of accurate control. Following studies that examine learning before convergence and under finite training budgets (Salimans & Kingma, 2016; Wu et al., 2021), and to avoid ceiling effects (Zhou et al., 2022), we use this paradigmatic reaching task for this comparison. In a simple task, prolonged training drives controllers toward very low error, leaving little room to reveal the teacher's contribution. We chose 700 updates as a common point after substantial learning: median task-only training error has fallen by more than 97% in all settings, yet residual error remains.

As intended by this design, task-only controllers are still improving at 700 updates. Training to 2,000 updates removes a further median 95.2–97.1% of the remaining error for GRU 128 and 77.2–85.4% for the Transformer. Even late in GRU 16 training, error keeps declining: in Monkey 1, comparing each run's median error over updates 8,000–8,950 with that over 9,000–10,000 gives median paired reductions of 14.3% (trained) and 13.4% (student-held-out targets). This is precisely the learning regime in which we ask whether neural supervision helps.

Neural supervision still helps late in training. In GRU 16 (Monkey 1), the strength selected by late-window training error alone (α = 0.025) lowers held-out error over updates 9,000–10,000, with a 10.6% median paired reduction (exact sign test; Holm-adjusted p = 0.0281 across 27 strengths). After 20,000 PPO cycles (Monkey 2, GRU 128), all 20 positive strengths yield lower median errors than PPO alone; at the training-selected strength, reductions are 44.6%, 26.0%, and 44.3% on trained, held-out, and new targets.

This proof of concept motivates testing neural supervision in harder tasks where substantial residual error persists under extended training budgets.

AuthorsOpenReview ↗

Detailed responses (Part 2/2)

3. Standard regularization and noise-augmented training

Add standard regularization baselines and noise-augmented training as comparators for the robustness result.

Thank you for this suggestion. We added 3,300 GRU fits, testing six weight-decay strengths and five training-noise levels, with 100 seeds per setting and animal. These controls use the same architecture, matched initializations and target splits, and the same 700-update training budget. We evaluate them under the original sensory-noise protocol.

The results reveal an interesting accuracy–robustness tradeoff, which we have integrated as a new, additional finding in the revised version of the manuscript:

  • Neuro-Dist has lower mean error under clean feedback and at the lowest positive test-noise amplitude than every tested conventional setting in all three animals.
  • At higher noise, weight decay and noise augmentation can achieve lower error, with a cost to clean accuracy. For example, augmentation with training-noise SD 0.05 reduces held-out mean RMSE at test-noise SD 0.1 by 41% relative to Neuro-Dist, while increasing clean RMSE by 135%. These percentages compare equally weighted dataset means.

Thus, cortical supervision improves accuracy and noise tolerance without noise-augmented training, while conventional robustness training can provide additional advantages at high noise. This motivates a next experiment combining Neuro-Dist with noise augmentation or weight decay to test whether their benefits can be combined while preserving clean accuracy. We now discuss this next step explicitly in the main text; it remains a proposed experiment.

The methods and results are reported in Appendix C.1, “Conventional regularization and noise-augmented training,” and Table 4, with a summary in the main-text robustness section.

4. Direct low-tangling regularization and mechanism

Does a direct low-tangling regularizer reproduce the gains? That would test whether tangling is the mechanism or merely correlated with it.

We particularly appreciate this suggestion, which prompted an intervention that substantially strengthens the mechanistic investigation. We trained GRUs with a direct tangling penalty and, as an additional control, a temporal-smoothness penalty. Across three animals, 100 seeds, and 44 tangling or 40 smoothness strengths, this adds 25,200 fits. The penalties use the full GRU state and only the training reaches, without a neural teacher. Strengths are selected by training MSE and then fixed for evaluation.

Direct tangling regularization reproduces part of the accuracy benefit: it reduces median clean reaching MSE relative to task-only training by 9.3–19.2% across all nine animal–target comparisons, covering trained, student-held-out, and entirely new targets. Neuro-Dist achieves larger gains, with lower median MSE in eight of these nine comparisons and at every tested positive sensory-noise amplitude in all three animals. At the highest tested noise level, its median MSE is 41–63% lower than that of direct tangling regularization. Neuro-Dist also generally outperforms temporal-smoothness regularization.

These results provide additional support for the utility of low tangling, extending the original correlational evidence. They strengthen our hypothesis that reduced tangling contributes to Neuro-Dist's benefits as one facet of a broader transfer of computationally useful neural population structure. The direct penalty's gains and the additional benefits of cortical alignment therefore support both parts of our original interpretation: tangling helps, and additional population structure may also contribute.

We have integrated these new key findings into Appendix F, “Direct tangling and temporal-smoothness regularization,” and Table 5, and revised the Discussion (Section 5) accordingly. Figure 13 additionally illustrates how the GRU trajectories evolve during matched task-only and direct-tangling training.

We want to thank the reviewer again for suggestions that have led to these new experiments and additional important findings!

Thank you for your responses. I maintain my score and would be happy to see this paper accepted.

Reviewer_QimkOpenReview ↗
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Informativeness
3
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Paper summary

The authors introduce a neural distillation paradigm for corticomotor data, and show that on a pooled dataset that contains three Macaques performing reaching tasks, corticomotor dynamics provide the controller with several benefits. Interestingly, the neurodist method is bested (when it is bested at all) only by a supervised behavioral baseline, which is a rather strong control, thus making this a very nice result. In addition to the reaching task, the authors also test the controllers in generalization and noise robustness experiments, demonstrating in both cases that neurodist beats other controls except for the behavioral control. I believe the experiments were statistically rigorous and carefully chosen.

The important contribution here is the novelty of applying the neural distillation paradigm, which is a prescient topic in NeuroAI, to motor tasks. Existing research primarily focuses on language or vision, with the exception of some very recent work.

Critical strengths

This paper has several critical strengths.

  1. The novelty in application of neural distillation to a motor task. Systems neuroscience has revealed very concrete computations conserved across species in motor control, which make it a prime target for the NeuroAI question of whether the constraints of this data provide useful inductive biases to artificial controllers. This question has been approached in other brain areas where the benefits of neural distillation are less clear and empirically shown little success, especially in language.
  2. Its use of publicly available primate data. In computational neuroscience, it is a very valuable if scientific progress to be made by the use of public datasets. Animal experiments are incredibly exhausting, expensive, and impose harsh conditions on the animals themselves. Thus, the fact that the authors leveraged existing datasets is both the ethical, efficient, and forward looking choice which should always be made by computationalists when such data can be used to support their scientific questions. This paper is a nice example that there is still plenty of insights to be gained from existing datasets in the context of neural distillation.
  3. The paper itself is very well written, with a logical progression of experiments that slice away at the interesting questions. The paper makes good use of its citations and motivates the work very clearly.
Critical weaknesses

There are a few minor things that could be improved.

1). There are a few recent works that also tackle corticomotor distillation, but these papers were not included in the authors positioning of their paper. Although I do believe this paper is a novel contribution, its main selling point hinges on the specific novelty being its application in motor. So, in order to justify this, the authors should adjust the intro/related works to account for how exactly their contribution differs from those cited below, and potentially adjust the phrasing to the specific contributions within the application of neural distillation to motor areas rather than the blanket application itself.

2). While I agree that the choice of CCA-based subspace alignment is well motivated by prior work, the authors should still have tested other alignment techniques given that these techniques have not yet been tested in motor cortex. It would be ideal to understand if CCA's role in model distillation is conserved across areas, or if there is another metric that might serve neurodist better. So beyond the precedent of CCA, is there something to be gained by specifically interrogating CCA. And the answer may very well be "no", but it would be useful for the authors to either 1) provide specific mathematical or empirical reasons beyond beyond the precedent of prior work for using CCA, or 2) provide ablation/alternative experiments that test different metrics.

3). Can you clarify why the behavior baseline beats the task baseline? It does not make sense to me why the task-optimized agent, given the simplicity of this task, would do worse than the behavioral distillation baseline. Also, why was the behavioral baseline chosen to be 4PCs with 5 temporal offsets? Seems arbitrary.

Questions for authors

My questions are described in the weaknesses, so please refer there.

5 comments
AuthorsOpenReview ↗

Detailed responses (Part 1/3)

Dear Reviewer Qimk,

Thank you for the insightful and constructive review. We are glad about the positive assessment of the experimental design, statistical analyses, and use of publicly available primate data. The comments and suggestions have helped us substantially improve the paper: they prompted a more precise account of the contribution, an extensive comparison of alignment objectives, and a clearer explanation of the behavioral control and training regime. The new alignment experiments also revealed an alternative alignment objective that can improve performance. We have incorporated all these new findings into the revised manuscript and supplement and respond to each point below.

1. Positioning relative to prior neural-supervised motor models

the authors should adjust the intro/related works to account for how exactly their contribution differs from those cited below, and potentially adjust the phrasing to the specific contributions within the application of neural distillation to motor areas rather than the blanket application itself

We agree that the contribution should be stated more precisely. Neural-supervised models have an established history in motor neuroscience, and our study builds on that history.

Unfortunately, the works the reviewer refers to as "cited below" do not appear in the review as we received it. We would be grateful if the reviewer could share these references, so that we can address each of them specifically in the revision.

In the meantime, we revisited the relevant literature and added Appendix J, "Extended related work: neural supervision, motor control, and control teachers," and Table 13, with a cross-reference from the main related-work section. The expanded discussion covers seven studies and distinguishes each study's scientific question, use of neural information, and findings. All seven address neuroscientific questions: they use trained networks to understand biological computation. All seven also use recurrent networks. None aims to improve the task performance of artificial controllers, including Transformers, relative to conventional training without neural supervision. Table 13 makes this distinction explicit in a new column, "Neuroscience or better AI/controllers?". Briefly:

  • Arai et al. (1994) ask how superior-colliculus dynamics and feedback generate saccades, fitting recurrent weights to recorded collicular neuron profiles.
  • Russo et al. (2018) ask why motor-cortex activity is not muscle-like and identify low trajectory tangling as a source of noise robustness. Their constrained networks follow synthetic or muscle-derived, rather than recorded, trajectories.
  • Russo et al. (2020) ask what population geometry is needed to track progress through an action. They embedded recorded supplementary-motor-area and motor-cortex trajectories into autonomous RNNs and examined how reliably these were reproduced under noise.
  • Cohen et al. (2020) ask how prefrontal populations select relevant inputs during context-dependent decisions, fitting recorded frontal-eye-field units together with a choice readout.
  • Sourmpis et al. (2023) ask which circuits generate trial-to-trial co-variability of neural activity and behavior, and contribute a trial-matching method for fitting spiking networks.
  • Almani et al.'s nuSim (2025) asks how embodiment and sensory feedback shape motor-cortical dynamics. It fits a subset of recurrent units one-to-one to recorded motor-cortex firing rates at the training speeds. At held-out cycling speeds, the network then matches the same neurons more closely than its unconstrained counterpart, while its kinematic error is not lower.
  • Zhou et al. (2026) ask how cortical dynamics support reliable choices together with variable, adaptable movements. They fit mouse cortical calcium activity and locomotor velocities in closed-loop navigation agents; agents fitted to individual trials adapt better to new obstacles than agents fitted to trial-averaged targets after additional readout training. We explicitly credit this behavioral result.

In contrast, our central Neuro-AI question is whether recorded cortical population structure can be used to improve an artificial controller's task performance. We address it through population-level auxiliary supervision of GRU, Transformer, and state-space controllers, as well as a PPO-trained policy (Appendices O–P), during reaching, with matched task-only and alternative-teacher comparisons, evaluations of reaching generalization, and sensory-noise robustness tests.

Raising this point thus has improved both the completeness of the related work discussion and the precision of our contribution statement. As mentioned above, if any other relevant prior study should have escaped our attention, we would be very grateful if you could point us to these studies, too.

AuthorsOpenReview ↗

Detailed responses (Part 2/3)

2. CCA and comparison to alternative alignment objectives

it would be useful for the authors to either 1) provide specific mathematical or empirical reasons beyond the precedent of prior work for using CCA, or 2) provide ablation/alternative experiments that test different metrics.

We thank the reviewer for this suggestion and have happily done both.

Why we chose CCA a priori. We selected CCA at the start of the project for three reasons beyond its successful use in brain-guided learning and model distillation (e.g., Pirlot et al., 2022). The Discussion (Section 5) states the physiological and practical reasons; Appendix I now adds the mathematical rationale:

  • Physiological: during reaching, heterogeneous motor-cortical neurons form organized, low-dimensional population trajectories (Churchland et al., 2012). CCA reveals the latent dynamics shared across recording sessions (Gallego et al., 2020) and across animals (Safaie et al., 2023), and these shared dynamics support movement decoding. CCA thus targets precisely the shared, behaviorally relevant population structure we aim to transfer.
  • Mathematical: CCA identifies shared linear population components after covariance normalization within each population. It is therefore invariant to rescaling and invertible linear mixing of units within either population; ridge regularization makes it well defined for our rank-four teacher stored in 12 coordinates.
  • Practical: CCA accommodates different population sizes and requires no correspondence between recorded neurons and artificial units, so the same objective applies to GRU and Transformer students.

Ultimately an empirical question. We fully agree that these reasons do not show that CCA is the best objective. We therefore compared CCA with five alternatives: normalized Procrustes alignment, linear centered kernel alignment (CKA), and distance-based (RKD-D), angle-based (RKD-A), and combined (RKD-D + 2 RKD-A) relational knowledge distillation. All use the same cortical teacher, GRU or Transformer students, seed-specific initializations and target splits, and the 700-update budget. Each objective was tested at 26 none-zero alignment strengths plus a shared task-only baseline, with 100 seeds per setting in each of the three animals: 93,600 positive-strength fits and 600 task-only fits. Strength was selected by median training MSE and then fixed for trained, student-held-out, and new-target evaluation.

Results: CCA was a good a priori choice, but better alternatives can exist.

  • CCA has lower median MSE than task-only training in all 18 animal–architecture–target-set comparisons, and the lowest median of all six objectives in 12 of them. It outperforms Procrustes, linear CKA, and angle RKD in all 18.
  • CCA is the only objective that selects a none-zero alignment strength in all six architecture–animal settings. Procrustes selects zero, i.e., no alignment, in five of six; for the Transformer in Monkey 1, all five alternatives select zero.
  • Distance RKD has the lowest median in the remaining six comparisons: GRUs in Monkeys 2 and 3, across all three target sets. In Monkey 2, it reduces GRU student-held-out MSE from 31.97 mm² with CCA to 20.02 mm², and new-target MSE from 29.57 to 19.21 mm².

Revision. The new Appendix I reports the objectives and their losses (Table 10), accuracy (Table 11), selected strengths (Table 12), and training error across strengths (Figure 17). Regarding the reviewer's question whether CCA's role is conserved across brain areas: we are currently running further experiments on this topic. We also consider this a very encouraging direction for future work and thank the reviewer again for bringing this topic up.

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Detailed responses (Part 3/3)

3. Behavioral control performance and design

Can you clarify why the behavior baseline beats the task baseline? [...] Also, why was the behavioral baseline chosen to be 4PCs with 5 temporal offsets? Seems arbitrary.

We thank the reviewer for raising these questions, which we agree were not sufficiently addressed in the original manuscript. The behavioral control is indeed strong: it has lower median error than task-only training in all 18 comparisons of Table 1, and wins 8 of 18 against Neuro-Dist's 10.

Why Behavior beats task-only training. In our interpretation, two reasons complement each other:

  1. A shared, finite training budget, by design. Following studies that examine learning before convergence and under finite training budgets (Salimans & Kingma, 2016; Wu et al., 2021), and to avoid ceiling effects (Zhou et al., 2022), we use this paradigmatic reaching task to test whether supervision improves the acquisition of accurate control within a shared budget of 700 updates; the revised main text now states this explicitly. In a simple task, prolonged training drives all controllers toward very low error, which would mask differences between teachers. At 700 updates, task-only controllers have reduced their initial training error by a median 98.8–98.9% (GRU) and 99.9% (Transformer), but are still improving: training to 2,000 updates removes a further 95.2–97.1% (GRU) and 77.2–85.4% (Transformer) of the remaining error (new Appendix H, Figure 14).

  2. Sparse task loss versus dense movement supervision. The task loss penalizes fingertip-to-target error only over the final 15 of 40 frames. It specifies where the hand must end up, not how to get there. The behavioral teacher aligns hidden states with recorded position and velocity structure at all 40 time points: a dense, trajectory-wide signal about how successful reaches unfold. Such auxiliary supervision can guide representation learning and speed up optimization.

Our control teachers support this interpretation. They add the same kind of dense alignment signal, but without reach-specific content. If any such signal helped simply as a regularizer, they should help similarly. They do not: the Shuffled teacher preserves the cortical trajectories and their time course but assigns them to the wrong reaches, and it is even worse than task-only training in some settings (e.g., Transformer, Monkey 1: 39.40 vs. 24.29 mm² on trained targets). Gaussian teachers matched to the cortical covariance spectrum, and synthetic Poisson teachers, generally yield smaller gains than Behavior, and Neuro-Dist significantly outperforms all three in aggregate comparisons (Appendix G). The largest gains arise only when the dense signal correctly describes each reach, as for Behavior and Neuro-Dist. This is expected if the teacher guides how each reach unfolds. Consistently, an exploratory analysis of GRU 16 controllers in Monkey 1, trained for 10,000 updates with the strength reselected for this late regime, found a remaining Neuro-Dist benefit: held-out error was lower in 65 of 100 seeds, with a median paired reduction of 10.6% (Appendix H.2, Figure 16).

Why four PCs and five temporal offsets. We have added a comprehensive design rationale as Appendix A.1 and Table 3. In brief, these settings were chosen based on the logic of the control, and were not tuned on outcomes:

  • Same variables: hand position and velocity, exactly those used to select the cortical subspace.
  • Four PCs match the cortical teacher's rank. Behavior thus differs from Neuro-Dist in content, not in dimensionality, alignment objective, or the 12 stored coordinates. Four PCs retain 89.25%, 97.88%, and 98.97% of the standardized feature variance in Monkeys 1–3, so little information is lost.
  • Five offsets (−100, −50, 0, +50, +100 ms) evenly cover a symmetric 200-ms window around each sample. This reflects heterogeneous neural–kinematic leads and lags of about 100 ms: motor-cortical activity can precede velocity by approximately 100 ms (Paninski et al., 2004) and relates to both preceding and subsequent movement (Takei et al., 2018).
  • Representation family. Instantaneous, time-delayed, and quadratic representations were compared in preliminary experiments. The time-delayed family was then frozen across animals, architectures, seeds, and strengths.

Future offsets are used only offline; deployment requires neither recordings nor future observations. The behavioral control is thus deliberately strong: it measures how much benefit recorded movement structure alone provides when dimensionality and alignment are matched to the cortical teacher.

We want to thank the reviewer again for these suggestions that led to a much clearer explanation of the behavior control design in the revised version of the manuscript.

Reviewer_4tbfOpenReview ↗
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Confidence
3
Informativeness
3(+2)
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1
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Paper summary

The paper proposes Neuro-Dist, which uses recorded macaque motor-cortical activity as high-dimensional training target for artificial motor controllers. Neural recordings are reduced through PCA and projected into a four-dimensional subspace selected by linear regression onto hand position and velocity. During training, a regularized CCA objective encourages controller hidden states to align with these fixed neural trajectories, plus a reaching-error objective. The authors evaluate a closed-loop GRU and an open-loop Transformer controlling a differentiable two-joint, six-muscle simulated arm using teachers constructed from three macaque datasets. Comparisons include task-only training, behavioral and engineered teachers, synthetic random teachers, and shuffled neural trajectories. They report improved reaching accuracy in aggregate, benefits on additional target directions, and improved sensory-noise robustness for GRUs. Reduced hidden-state trajectory tangling is presented as a possible mechanism.

Critical strengths

The experimental controls meaningfully test whether the teacher’s structure matters. The comparisons extend beyond task-only training to include smoothed Gaussian signals, synthetic Poisson activity, shuffled neural trajectories, an engineered directional representation, and a behavioral PCA teacher. Applying these through the same alignment objective helps distinguish the value of a particular teaching representation from the mere presence of an auxiliary loss. The behavioral teacher is an especially relevant and substantive comparison.

Critical weaknesses

The source of the advantage over non-neural supervision remains insufficiently isolated. The neural teacher is explicitly selected for its linear relationship with hand kinematics, so it is important to establish what useful information it contributes beyond a suitably constructed low-dimensional behavioral representation (e.g. the Behavior baseline is competitive). Moreover, the authors acknowledge that the behavioral baseline does not match the neural teacher’s covariance spectrum or effective alignment gradients. Since the alignment objective uses regularized CCA, these differences leave open explanations involving representation conditioning or regularization properties rather than uniquely useful cortical activity structure. Better matched behavioral or engineered teachers, and comparison with direct temporal smoothness or tangling regularization, would strengthen their interpretation.

Questions for authors

How sensitive are the results to the construction of the neural representation? The teacher depends on smoothing, averaging, PCA, and selection of a behavior-predictive subspace. How robust are the gains to the retained dimensionality and smoothing scale? Would unselected neural PCs or random neural subspaces provide similar benefits?

How far do the benefits generalize beyond the current reaching setup? Could you evaluate different initial postures, target distances, physical perturbations, or arm and muscle parameters? Such tests would clarify whether the teacher transfers broadly useful control structure despite the absence of a demonstrated match between simulated and macaque biomechanics.

Does the method remain beneficial with simpler controllers or different training algorithms? The GRU already provides a per-step feedback controller, but a simpler controller with an explicit low-dimensional state would help assess the necessary complexity. Would neural alignment also improve a policy trained with other methods such as reinforcement learning?

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Overview of the revision

Dear Reviewer 4tbf,

Thank you for the insightful, constructive, and positively challenging review. Its questions concern the very core of the neuro-distillation methodology and answering them thus required substantial new work, which has considerably deepened our understanding of when and why neural supervision helps.

Overview of the revision. Addressing the reviewer's questions led to:

  • six new dedicated appendices (K–P) and a new section reviewing control teachers in the literature (J.4);
  • two new subsections on reduced-capacity and extended training (H.1–H.2);
  • a new main-text Figure 2, illustrating what a neural teacher looks like;
  • a new Results paragraph on state-space and reinforcement-learning controllers, with an updated Discussion.

Each answers a specific question from the review. We summarize the main findings here; the following five comments answer each point in detail.

1. How the teacher is constructed (Appendices K–M): The benefit does not critically depend on the original construction.

  • A simpler and more general Neuro-Dist variant. The reviewer's question about unselected neural PCs directly led to a very practical improvement of the method. Teachers built from the leading neural PCs alone, selected by neural variance without any kinematic data, perform at least as well as the original construction: among five methods, the leading four PCs have the lowest median error in 9 of 18 comparisons; leading two PCs give the largest aggregate reductions (47.0% student-held-out, 43.2% new targets); and leading-PC teachers take the four best positions in pooled physical generalization (19.6% below task-only, versus 15.9% for the original). Neuro-distillation therefore no longer requires behavioral recordings to define its teacher subspace.
  • Random neural subspaces also help, but less: they improve on task-only training in 17 of 18 comparisons, with smaller aggregate reductions than the leading four PCs (38.7% vs. 44.8% student-held-out, 31.7% vs. 40.8% new targets).
  • Halving or doubling the smoothing width preserves the benefit in all 18 comparisons at every width.
  • With matched covariance, all nine aggregate comparisons favor neural over behavioral trajectories.
  • Two further experiments testing trial averaging and upstream PCA retention are running; we will report them shortly.

2. Teacher controls (Appendix J.4). We expanded the alternatives from five to 18 teacher variants (neural subspaces, covariance transforms, preprocessing), with complete alignment-strength sweeps. Teacher-free controls add conventional regularization, noise augmentation and direct geometric penalties.

3. What is transferred (Appendices E–F, I, M). A direct tangling penalty reproduces part of the benefit, reducing error by 9.3–19.2%, but Neuro-Dist remains better in eight of nine comparisons. Neither covariance matching nor smoothness penalties account for the full effect. This sharpened our interpretation: neural population trajectories act as a structured training prior, of which low tangling is one, but not the only factor.

4. Generalization (Appendix N). We evaluated 1,800 frozen controllers in 67 physical scenarios, varying initial posture, target distance, curl forces, muscle strength and limb inertia. Pooled across all scenario families, Neuro-Dist has the lowest error of the three original methods, 15.9% below task-only training and narrowly ahead of Behavior. Family profiles also show where it does not help: at target distances away from the trained 10-cm radius and under curl-field forces.

5. Controllers and training algorithms (Appendices H, O, P). Neural supervision also improves a 16-state GRU with 97% fewer parameters, a state-space controller (42.7–51.3% lower student-held-out error), and a PPO-trained policy after 20,000 cycles (26.0–44.6% lower error across target sets).

Checking our own controls against the literature. The reviewer's emphasis on rigorous controls also prompted us to ask whether we had overlooked any established control. We therefore reviewed how 24 study families using neural supervision construct alternative teachers (Appendix J.4). The review confirmed that our shuffled, statistical and behavioral controls correspond to constructions used in the field. For context, individual studies include up to three alternative-teacher constructions, and one reports complete strength sweeps for them. As a direct result of the reviewer's questions, our study now includes 18 alternative teacher variants, each with complete strength sweeps. Together, they show which properties of the neural teaching signal drive the benefit and how this benefit depends on alignment strength.

We are grateful for the time and care the reviewer invested. Their questions have made this a much more carefully controlled study, and we hope the revision addresses their concerns.

AuthorsOpenReview ↗

Detailed responses (Part 1/2)

In the following, we describe the new experiments and findings summarized in our overview in more detail.

1. Sensitivity to the construction of the neural teacher

How sensitive are the results to the construction of the neural representation? [...] Would unselected neural PCs or random neural subspaces provide similar benefits?

Unless stated otherwise, all new experiments here and below use the three animal datasets, GRU and Transformer controllers, 100 seeds per setting and the original 700-update budget. Alignment strength is selected on training error and then fixed for student-held-out and new-target evaluation. Aggregate reductions are equal-weight geometric means of the six animal/controller median-MSE ratios relative to task-only training.

Subspace selection (Appendix K.1, Figure 19). We replaced the kinematics-selected teacher with the leading four PCs or a random rank-four subspace of the same 12-dimensional neural parent. Random projectors are sampled per animal and seed, not selected by performance. Both improve on task-only training in 17 of 18 comparisons. Leading four PCs and original Neuro-Dist split their direct comparisons 9–9; original Neuro-Dist outperforms the random subspace in 12 of 18.

Teacher rank (Appendix K.2, Figure 20). Ranks one to four reduce student-held-out error by 43.6%, 44.0%, 45.8% and 44.8%, and new-target error by 37.3%, 41.2%, 42.2% and 40.8%. No single rank is uniquely optimal.

Lower-variance components (Appendix K.3). The leading two PCs reduce student-held-out/new-target error by 47.0%/43.2%, PCs 11–12 of the retained parent by 26.3%/19.2%, and the two lowest nonzero PCs of the full recorded populations by 35.0%/30.7%. Useful supervision thus extends beyond the leading PCs, which help most.

Smoothing (Appendix L, Figure 21). We re-smoothed the spike rates with Gaussian SDs of 15, 30 (original) and 60 ms and refitted the complete teacher pipeline. Student-held-out reductions are 47.7%, 44.1% and 42.1%; new-target reductions are 38.4%, 39.9% and 36.3%. Every width improves on task-only training in all 18 comparisons.

Trial averaging and upstream PCA retention are being tested in two running experiments (31,200 fits each): teachers built from 25%, 50% or all trials, and from 6, 12 or 24 upstream PCs. We will report both in a follow-up comment.

2. Control teachers and strength dependence

The comparison now includes 18 alternative teacher variants, up from five (Appendix J.4, Table 16): the five original controls (Behavior, Ring, Gaussian, Poisson, Shuffled), seven neural-subspace variants, four covariance transforms and two smoothing widths.

Full alignment strength sweeps are reported for every comparison: 40 none-zero alignment strengths for the original controls, 21 or 26 for the subspace comparisons, 21 for covariance and 26 for smoothing. The covariance analysis additionally separates strength selection from evaluation across seed folds. The sweeps show how gains depend on strength, including where strong alignment hurts. Teacher-free controls (weight decay, noise-augmented training, direct tangling and temporal-smoothness penalties) complement these teacher comparisons.

3. What structure is transferred?

Low tangling as a transferred feature (Appendices E–F). Neuro-Dist reduces median GRU training tangling by 48–68% without an explicit penalty. A direct tangling penalty improves reaching error by 9.3–19.2% in all nine animal/target-set comparisons, providing additional evidence for its usefulness. Neuro-Dist, however, remains better in eight of nine comparisons and has 41–63% lower error at the highest sensory-noise level, and temporal-smoothness penalties also fall short.

Covariance alone does not explain the advantage over Behavior (Appendix M, Figure 22). Across three covariance treatments, all nine aggregate comparisons favor neural over behavioral trajectories. Under common whitening, reductions relative to whitened Behavior are 24.1%, 18.7% and 11.4% on trained, student-held-out and new targets; the trained-target contrast survives the nine-test Holm correction (p = 0.0234). Even at matched covariance, the two sources produce different alignment gradients.

Interpretation. These results point to that what is transferred is the condition-specific organization of neural population trajectories, that is, how population activity unfolds for each movement, rather than any single summary statistic. This structure survives changes of subspace, smoothing and alignment objective. It is not fully reproduced by matching covariance, by penalizing tangling or roughness, or by shuffling trajectories across movement conditions. Low trajectory tangling is one measurable factor contributing to the neuro-distillation benefit; investigating further potential factors would be a natural next question.

(Continued in Part 2/2.)

AuthorsOpenReview ↗

Detailed responses (Part 2/2)

4. Generalization beyond the training setup

How far do the benefits generalize beyond the current reaching setup? Could you evaluate different initial postures, target distances, physical perturbations, or arm and muscle parameters?

We completed all four requested types of test (Appendix N, Figures 23–24, Tables 28–29). The best-generalizing controllers are all neural teachers. In an expanded comparison of 16 methods and 9,600 frozen controllers, the leading-three-PC teacher has the lowest pooled error index, 0.804 (19.6% below task-only training); leading-PC teachers of rank one to four occupy the four best positions, followed by original Neuro-Dist. Leading one and two PCs even improve the distance average, by 4.3% and 3.6%.

Evaluation design. Controllers were evaluated in 67 physical scenarios, giving 120,600 rollouts for the original three methods, each covering all 36 directions. No retraining, strength reselection or neural supervision occurs during evaluation. The pooled index geometrically averages error ratios to task-only across seven families: five physical families plus student-held-out and new directions, weighting families, levels and animal/controller cells equally.

Original three methods. Pooled indices are 0.841 for Neuro-Dist, 0.849 for Behavior and 1 for Task-only. Physical-family ratios (lower is better):

InterventionNeuro-DistBehavior
Initial posture, ±10° per joint0.8270.792
Target distance, 4–14 cm1.2891.203
Curl forces, ±2 to ±16 N·s/m1.2761.228
Muscle strength, ×0.8–1.20.8040.813
Segment mass/inertia, ×0.8–1.20.7880.794

Angular generalization reduces error by 43.3% (student-held-out) and 39.2% (new directions), compared with 39.9% and 30.1% for Behavior. Both teachers improve reaches at 9 and 11 cm, adjacent to the trained 10-cm radius, whereas farther distances and curl fields favor task-only training. Thus, neural supervision learned at a single nominal setup transfers, without any retraining, to new directions, initial postures, muscle strengths and limb inertias. Pooled over all families, Neuro-Dist generalizes at least as well as Behavior, and teachers built from leading neural PCs generalize best overall. Notably, this transfer arises even though the simulated arm was never matched to macaque biomechanics.

5. Controller complexity and training algorithms

Does the method remain beneficial with simpler controllers or different training algorithms? [...] Would neural alignment also improve a policy trained with other methods such as reinforcement learning?

Compact controllers (Appendix H.1–H.2, Figures 15–16). Task-only GRUs with 16, 32 and 64 states all learn the task. GRU 16 has 1,734 parameters, versus 56,838 for GRU 128, and its state is 16-dimensional throughout training and deployment. Trained for 10,000 updates on Monkey 1 across 27 strengths, GRU 16 with the strength selected by late-window training error (α = 0.025) lowers student-held-out error in 65/100 seeds, with a 10.6% median paired reduction (exact sign tests, Holm-adjusted p = 0.0281).

Structured recurrence (Appendix P, Figures 27–28, Table 31). A state-space controller with a learned diagonal linear recurrence (64 complex states) and a nonlinear muscle readout tests a different state-update structure. Neural alignment reduces median student-held-out error by 42.7%, 44.3% and 51.3% in the three datasets. Neuro-Dist outperforms Ring in all three datasets and Behavior in two.

Reinforcement learning (Appendix O, Figures 25–26, Table 30). We trained 2,100 PPO policies: a GRU 128 actor on Monkey 2, with 100 seeds at each of 21 strengths, for 20,000 cycles. Neural alignment adds a CCA term on the actor's hidden states, without gradients through the simulated arm. At the alignment strength selected by training error:

Target setPPO alone (mm²)PPO + Neuro-Dist (mm²)Reduction
Trained71.4739.5944.6%
Student-held-out69.7451.6026.0%
New directions74.6341.5544.3%

All 20 none-zero alignment strengths improve all three final medians, and learning curves show lower errors under neural supervision over much of later training. This experiment establishes a first step to extend neuro-distillation also to reinforcement-learning-based policies.

Together, these results show that the benefit extends across recurrent capacity, state-update structure and learning algorithm, within the tested reaching task. We want to thank the reviewer again for raising this set of topics and questions, addressing which substantially shaped an dimproved the revised version of the manuscript.

Comments on the paper

1 comment

Dear Reviewers and Area Chair,

We sincerely thank all three reviewers and the Area Chair for the time, care and thought invested in evaluating our work. This was an exceptionally constructive and fruitful review process. We are encouraged by the closing feedback:

  • 4tbf has raised their score from 2 to 3. They find the six-PC teacher results convincing, the cross-animal frozen-controller results encouraging, and express particular interest in the direction-dependent rotational-plane findings.
  • Qimk confirms that the revised related work and our responses on alignment metrics and the behavioral control satisfy their remaining concerns, and recommends acceptance.
  • 9Xdu maintains their score and states that they would be happy to see the paper accepted.

The rebuttal has made this a substantially deeper and stronger paper. The expanded study combines extensive control and sensitivity experiments with broader generalization tests and a more detailed investigation of which neural population structures are transferred to artificial controllers.

For convenience, the main new or expanded supplementary sections are summarized below:

Supplement sectionAdditionReviewer comments
A.1Behavioral-teacher design rationaleQimk
C.1, FConventional robustness controls; direct tangling and smoothness penalties4tbf (F), 9Xdu
HConvergence, extended training and reduced-capacity controllers4tbf, Qimk, 9Xdu
I, MAlternative alignment objectives and cortical sourcesQimk
JRelated work, contribution positioning and control-teacher literature4tbf, Qimk
K–LNeural subspaces, dimensionality and preprocessing sensitivity4tbf
NCovariance-matched neural and behavioral teachers4tbf
O, RPhysical generalization and cross-animal evaluation of frozen controllers4tbf
P–QReinforcement-learning policies and state-space controllers4tbf
S–TTransferred population geometry and direct movement-plane interventions4tbf, 9Xdu

Our latest follow-up to 4tbf additionally reports cross-animal teacher transfer during fresh controller training, complementing the frozen-controller evaluations in Appendix R.

Integration of the extensive new material into the main text is ongoing, with particular emphasis on explaining the biological and theoretical meaning of the geometric findings, as 4tbf recommends. Detailed results are available in the supplement and our follow-up replies. To make the successive revisions easy to follow, changes in the last three revision stages are marked in blue, green and turquoise, respectively, from earlier to latest additions.

We are sincerely grateful for this discussion and for the opportunity to improve the study. It has helped us develop a more carefully tested first systematic account of when and how neural population structure can be leveraged to improve artificial control in recurrent networks and transformers, through neuro-distillation.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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