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Withdrawn from ICLR 2027

Task Coverage or Repeated Exposure? A Study of Learning from Execution Feedback

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Task-set scaling in execution-feedback post-training changes both task coverage and repetition under a fixed budget, so nominal task count does not specify the training allocation. We study this problem with Qwen3.5-4B and group-normalized policy gradient (PG) on nested Structured Query Language (SQL) and arithmetic task sets of \(N=64\), \(256\), and \(1,024\). We compare rollout-count and generated-response-token endpoints, measure realized task coverage, generated tokens, updates, wall-clock time, and acquisition cost, vary task composition and reference complexity, and evaluate six adaptation methods on reserved final tasks under a registered 7,200-second pipeline budget. \(N=256\) gives the highest development mean, while \(N=1,024\) does not continue the gain and the original quantity endpoints are close on the reserved test. Rollout-count and token endpoints produce different exposure and cost, task composition and reference complexity change outcomes at fixed \(N\), and no tested adaptation method exceeds the unadapted checkpoint under the common time budget. These results establish that task-set scaling is a training-allocation claim: interpretation requires separating new task coverage from repeated feedback and accounting for endpoint and resource costs. This allocation diagnosis gives researchers a basis for deciding whether limited budget should purchase new tasks, repeated feedback, or further adaptation, and for judging whether an observed gain transfers when the budget or endpoint changes.

Primary area:
reinforcement learning
Keywords:
Reinforcement Learning, Large Language Models, Task-Set Scaling, Execution Feedback, Training Allocation

Reviews

Among:
Shape:
1234this paper, Bottom 2%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.33 over 3 reviews, above 2% of the others.
Reviewer_ohd2OpenReview ↗
Rating
1
Confidence
4
Informativeness
1
Presentation
2
Soundness
2
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Paper summary

The paper is about the trade-off between spending RL rollouts on the same task as compared to a diversity of tasks. Using Qwen3.5-4B with group-normalized on-policy policy gradient, the authors take two tasks (SQL and math) and fix the amount of rollouts the model is allowed to train with. They then vary the amount of each task type the model sees: 64, 256, and 1024. The experiments showed the best performance on the training set at 256, but that the differences were negligible on the test set. They also noticed that despite fixed rollouts, the actual amount of wall clock time and tokens used varies a lot based on the number of tasks. The key takeaway is that task set size in isolation is not a good metric of how to allocate training time.

Critical strengths
  1. Careful experimental design. As an empirical study, this paper is well designed and reports comprehensively. They report task coverage, generated tokens, active optimizer updates, wall-clock time, and acquisition costs rather than relying solely on task counts or rollout budgets. The comparison between rollout count and number of tokens shows how different budget definitions can lead to different experimental comparisons. This is a useful methodological contribution for evaluating execution-feedback post-training. I'm also happy they reported negative results with respect to the effect of the adaptation methods.
Critical weaknesses
  1. Limited insight into the central research question. The paper aims to understand how the allocation of a fixed training budget between task coverage and repeated exposure affects learning. The experiments show little difference on the test set, even in comparison to the base model (which is a little suspicious: we know broadly that RLVR works, so I suspect there's some training issue that is worth double-checking). Consequently, the experiments don't establish a clear or generalizable relationship between task allocation and downstream performance, nor do they provide much insight into when additional task coverage should be preferred over repeated exposure. The principal conclusions instead concern the importance of accounting for training costs and evaluation endpoints, which, while interesting, offer limited new scientific insight into the motivating question. If they were to make this a key contribution of the paper by pointing out this as a common issue in research, I would like a data-driven study of the literature.
Questions for authors
  1. The main positive finding is that N=256N=256 achieves higher SQL/GSM training accuracy. However, the reserved final evaluation uses GSM8K and MBPP, excluding SQL, which constitutes half of the training tasks. Could the authors clarify the rationale for this difference in evaluation domains? Is there independent held-out SQL evidence indicating whether the training set improvement generalizes?

  2. The three allocations achieve nearly identical performance on the test set, with none consistently improving over the base model. Why didn't the training change performance relative to the base model? Also, do the results indicate that the different allocations produce essentially the same predictions, or that different allocations do well on a statistically significantly different set of problems?

Reviewer_VRTCOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper investigates the trade-off between task coverage and repeated exposure in execution-feedback post-training under limited computational budgets. Using Qwen3.5-4B with group-normalized policy gradient, the authors construct nested SQL and arithmetic task sets of N = 64, 256, and 1,024, and compare training outcomes under fixed rollout-count and generated-response-token endpoints. The study further examines task composition, reference-solution complexity, transfer performance, and resource consumption, and evaluates six adaptation methods under a common training-time budget. The results show that N = 256 achieves the highest development SQL/GSM macro accuracy, while increasing task quantity to N = 1,024 does not provide further improvement. However, this advantage does not translate into a consistent gain on reserved final tests. Under the 7,200-second training budget, none of the six adaptation methods outperforms the unadapted checkpoint in mean final-test accuracy. The findings highlight the importance of distinguishing task quantity from realized exposure and resource costs, although the stability of the observed allocation patterns across different training budgets remains uncertain.

Critical strengths
  1. The paper distinguishes task-set size, realized task coverage, generated response tokens, optimizer updates, and wall-clock time. Section 4.3 and Figure 3 show that equal rollout counts can produce substantially different resource consumption, with generated tokens varying by approximately 3.19 times. The authors also report unavailable endpoints, failed runs, and individual seed results. This transparency strengthens the reliability of the empirical analysis and provides useful guidance for reproducible execution-feedback training studies.

  2. The study compares multiple task-set sizes and training endpoints, examines task composition and reference complexity, and includes reserved final tests and an unadapted checkpoint. The results reveal that development improvements do not necessarily translate into held-out gains, and that none of the six adaptation methods exceeds the base model under the fixed training-time budget. These findings provide useful evidence against evaluating training effectiveness solely through development accuracy or nominal task quantity.

Critical weaknesses
  1. Section 3.3 compares N = 64, 256, and 1,024 under a fixed total of 1,024 prompt presentations, corresponding to sixteen, four, and one presentation per task, respectively. This design appropriately examines the coverage-repetition trade-off under a fixed sampling budget. However, the observed preference for N = 256 is established primarily under a single rollout budget. Although the paper also evaluates a 500,000-response-token endpoint, this uses a different budget definition rather than systematically varying the budget. The relative benefits of coverage and repetition may change with the available training budget. Additional comparisons across different total rollout budgets would help establish whether the observed allocation pattern is stable or budget-specific.

  2. Section 4.1 and Figure 2 report that N = 256 achieves the highest development SQL/GSM macro accuracy of 88.54%, compared with 81.25% and 84.38% for N = 64 and N = 1,024. However, Table 3 shows much smaller differences on the reserved GSM8K/MBPP evaluation, with corresponding macro accuracies of 83.25%, 83.42%, and 83.17%. While the authors appropriately acknowledge that development gains do not consistently transfer, the paper does not provide sufficient statistical analysis to determine whether the small held-out differences reflect meaningful allocation effects or evaluation variability. Paired task-level comparisons and uncertainty estimates would strengthen the interpretation of the observed task-allocation patterns.

  3. The experiments use only Qwen3.5-4B and primarily study single-response SQL and arithmetic training tasks. Moreover, Section 3.2 states that the nested task sets are constructed from a single draw, with the three seeds varying training randomness rather than task selection. Therefore, the reported seed variability does not capture uncertainty across independently sampled task sets. The observed allocation patterns may differ across model scales, task distributions, or multi-turn execution-feedback settings. Broader validation would strengthen the generality of the conclusions.

  4. Section 5.2 compares six adaptation methods under a common 7,200-second training pipeline budget, providing a useful time-controlled evaluation. However, the reported pipeline budget excludes setup and final export, while RFT and DPO require an additional acquisition stage involving 4,096 attempts, 780,509 generated response tokens, and approximately 2,980 seconds. Although these acquisition costs are reported separately, they are not incorporated into a unified end-to-end resource comparison. Moreover, the paper does not provide matched total training-compute measurements, and Section 5.2 notes that FLOPs remain unmatched. Consequently, the relative efficiency of these methods under a complete resource budget remains unclear. An end-to-end comparison including acquisition and training costs would strengthen the paper's resource-allocation conclusions.

Questions for authors
  1. Section 3.3 compares task quantities under a fixed total of 1,024 prompt presentations and additionally considers a 500,000-response-token endpoint. Could the authors compare multiple total rollout budgets, or clarify whether the preferred allocation is expected to change as the budget increases? This would help determine whether the advantage observed at N = 256 reflects a general allocation pattern or a budget-specific result.

  2. Table 3 reports very similar reserved final-test accuracies across N = 64, 256, and 1,024, despite the larger development differences in Figure 2. Could the authors provide paired task-level comparisons or confidence intervals for these held-out differences? This would clarify whether the observed differences reflect reproducible task-allocation effects or evaluation variability.

  3. Section 3.2 states that all nested task sets come from a single task draw. Could the authors provide results from independently sampled task sets or quantify the potential impact of task-selection variability? This would clarify how broadly the observed allocation patterns can be interpreted.

  4. Section 5.2 reports a fixed 7,200-second training pipeline budget, while acquisition costs for RFT and DPO are accounted for separately. Could the authors provide an end-to-end comparison that includes both acquisition and training costs, or clarify how to interpret the reported efficiency conclusions when these additional costs are included? Such evidence would better establish the relative resource efficiency of the compared methods.

Reviewer_yjfNOpenReview ↗
Rating
1
Confidence
2
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

The paper studied a practical allocation promlem for limited-budget post-training, i.e., task coverage and repeated exposure trade off. The paper built nested SQL/arithmetic task populations with 64, 256, and 1,024 tasks; trained Qwen3.5-4B with group-normalized on-policy policy gradient.

Critical strengths
  1. The paper studied a practical allocation problem for limited-budget post-training. This is useful for designing and interpreting post-training experiments.
Critical weaknesses
  1. The study evaluates only one base model and two training domains, and does not assess the robustness of its conclusions across independently resampled training task sets.
  2. The paper provides neither confidence intervals for performance differences nor formal statistical significance tests. The current evidence is therefore insufficient to establish whether differences across task counts and training methods are robust, particularly the small differences observed on the final test set.
Questions for authors

Whether differences in task complexity could affect the results?

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