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Under review as a conference paper at ICLR 2027

Idol Learning: Probe Before Commit for Rare-Success Reinforcement Learning

Abstract

Rare successful trajectories can reflect either reproducible behavior or favorable environmental randomness. Directly reinforcing them risks consolidating lucky outcomes. We introduce Idol Learning, a probe-before-commit framework that treats a high-return trajectory as a behavioral hypothesis. After an ordinary learner update, Idol temporarily amplifies the trajectory's action likelihood, compares fresh reference and probe rollouts, and retains an evidence-dependent fraction of the same candidate displacement. This separates the strength of a diagnostic intervention from that of permanent learning. Under matched interaction budgets, controlled experiments show substantial gains with REINFORCE and earlier acquisition or improved final skill with PPO. Probe-strength sweeps distinguish useful temporary amplification from harmful unconditional commitment. However, stronger local masking reverses the gains: reward-based validation can accept updates that damage the intended skill. DeepSea shows earlier consolidation than successful-experience replay in a retrospectively selected discovery cohort; exploratory FrozenLake runs show higher mean online success with heterogeneous outcomes. These results support active validation of rare success when interventions expose informative behavioral differences, while identifying candidate construction, reward fidelity, and commitment calibration as limits to broader reliability.

Primary area:
reinforcement learning
Keywords:
reinforcement learning, sparse rewards, self-imitation learning, policy optimization, diagnostic interventions

Reviews

Among:
Shape:
1234this paper, Bottom 10%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_JZLwOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
3
Read review
Paper summary
  • This paper proposes Idol Learning, a framework which aims to solve the issue of sparse rewards updating models in the wrong way due to randomness. In their approach, they select the most promising updates against the trajectories with the highest rewards and amplify if it if succeeds in an follow-up test.
  • The authors find that Idol Learning can significantly improve performance against simple baselines in a controlled experimental setting tuning and in DeepSea and FrozenLake
Critical strengths
  • The general idea seems relatively novel and intuitive. The results in Figures 1 and 2 provide compelling evidence that this approach outperforms standard methods in a step-controlled setting.
  • Providing additional results in Figure 3c where the approach doesn’t work well gives extra understanding in where the method works well and poorly
Critical weaknesses
  • It is not clear how we can apply this approach in more complex domains. The authors only evaluated simple domains such as the synthetic controlled domain, and simple MDPs like DeepSea and FrozenLake. But in domains with much larger state spaces, creating an amplification which can regenerate this this in the testing might become difficult. The authors discuss this limitation for FrozenLake, but I believe this is a strong hurdle for successful implentation in any real-world domain where we might want to use this method because of the requirement for generating informative probes during validation.
Questions for authors
  • Can you provide additional experimental results in more complex and real-world domains where this approach could work?
1 comment

We thank the reviewer for highlighting the importance of scalability to complex environments. We agree that extending the framework to large-scale and real-world domains is an important direction for future research.

We would like to emphasize, however, that the primary contribution of this paper is to introduce and investigate a new learning principle, rather than to establish a general-purpose solution for complex RL environments.

The central insight of Idol Learning is that rare successful experiences should be treated as hypotheses to be tested before being reinforced. This motivates a new probe-before-commit framework that separates temporary behavioral amplification, used to evaluate a candidate update, from permanent policy commitment. We believe this conceptual distinction is valuable in its own right and opens up a different perspective on learning from rare successes.

Our experimental design is deliberately controlled to isolate and systematically investigate this principle. By separating genuine behavioral skill from favorable environmental randomness, we can directly examine when reinforcing rare successes is beneficial or harmful, why temporary amplification and permanent commitment should be treated differently, and what additional value active validation provides. These findings establish the motivation and empirical foundation for the proposed framework.

We fully acknowledge that constructing informative probes becomes more challenging as environments grow in complexity. Developing scalable candidate construction and efficient validation mechanisms is a substantial research problem in its own right, and we see it as a natural next step building on the framework introduced here.

Reviewer_YoXqOpenReview ↗
Rating
2
Confidence
2
Informativeness
1
Presentation
3
Soundness
2
Read review
Paper summary

Idol Learning temporarily amplifies a successful trajectory, evaluates the candidate policy through fresh rollouts, and retains part of the update based on the evidence.

Critical strengths

The probe-before-commit idea is interesting. The experiments account for validation interactions and transparently report failures.

Critical weaknesses
  • Comparisons do not establish an advantage over simpler alternatives, such as smaller imitation updates or KL-constrained updates.
  • Evaluation is limited to small environments. DeepSea highlights a selected discovery cohort, while FrozenLake lacks held-out-seed validation and independent final-policy evaluation.
  • Reliability and efficiency remain unclear: some settings show substantial degradation, partially committed policies are not directly validated, and probing consumes considerable interaction budget.
  • The font and heading styles appear inconsistent with the ICLR template.
Questions for authors

Can the authors compare against simpler conservative updates, provide independent benchmark evaluation, and report wall-clock overhead?

1 comment
AuthorsOpenReview ↗

Response to Reviewer YoXq

  1. Comparisons with simpler conservative updates

We added FR-08 (§4.3.1), comparing validated LB against six no-validation conservative commit rules (fixed fractions and KL constraints) under matched interaction budgets, with unused validation budget recycled into PPO training.

Across H = 5–8, validated LB achieves 99.99%, 99.98%, 79.95%, and 37.79% final skill, exceeding the best no-validation setting at each horizon (94.00%, 88.35%, 55.56%, and 21.98%). 41/48 multiplicity-adjusted paired intervals are positive across endpoint and AUC comparisons.

  1. Independent benchmark evaluation

We added 50 new held-out FrozenLake training seeds (§4.6), fixing all configurations before training and independently evaluating each frozen final policy over 2,000 episodes.

Mean success rates are 5.421% (Idol), 3.930% (SIL), and 3.005% (PPO). Idol improves over SIL by +1.491 percentage points (adjusted CI [0.029, 3.261]) and PPO by +2.416 points ([0.986, 4.121]).

  1. Reliability, partial commits, and overhead

We added FR-09 (§4.5.1), investigating smaller commits after LB validation. At local-mask q = 0.3 and 0.5, fixed-0.1 validated commits after LB gate with budget recycling improve final skill from 61.35% to 99.30% and 53.07% to 98.85%, respectively, with all 50 seeds reaching at least 90% skill in both settings.

Holding the commit fraction at 0.1, retaining LB validation outperforms removing it by 17.78–53.28 percentage points across q = 0.3, 0.5, 0.8, with positive adjusted intervals. These results substantially mitigate the original failures.The original experiments already accounted for probing costs through matched environment-step budgets: baseline learners spend all interactions on training, while Idol allocates part of the same budget to validation.

We also added wall-clock measurements (Appendix D.1.6), showing comparable runtime to PPO in the tested small-scale implementation. FrozenLake validation consumes 31.99% of the interaction budget, which we now explicitly report.

  1. Formatting

We corrected the font, heading styles, and title, and reorganized the algorithm (§3) and experimental setup (§4.1–4.2) for clarity.

We appreciate the reviewer's suggestions, which motivated these additional comparisons and independent evaluations.

Reviewer_Voa9OpenReview ↗
Rating
1
Confidence
3
Informativeness
1
Presentation
1
Soundness
1
Read review
Paper summary

The paper looks to prevent lucky successful trajectories from significantly affecting the policy optimization. The authors derive a probe-before-commit procedure that uses temporary policy interventions to evaluate additional updates proposed by rare successful experience before committing them. They perform experiments on sythetic domains.

Critical strengths

The setting is interesting. Preventing rare successes to skew optimization may be an interesting optimization problem.

Critical weaknesses

(1) The presentation is very bad. First of all, the style file used is different. This alone can be a valid reason for a rejection. Even if the style file was correct, there are still major concerns:

(a) The experiment setup is missing. There is mention of DeepSea and FrozenLake, which I didnt not find the citations to, so am not sure what they look like, what the problem is, what the prompts/responses/trajectories look like. Still, DeepSea and FrozenLake experiments are mentioned in section 5.4. What about all the previous experiments? What domain are they in?

(b) What does "Representative gates." mean in line 118? Seems very weird. Should it be a paragraph header or sub section? Otherwise it a two word sentance without any verb.

(c) The algorithm is missing. With a confusing method, atleast an algorithm box could help.

(d) The paper title in the pdf is "Idol learning" while in the submission is, "Idol Learning: Probe Before Commit for Rare-Success Reinforcement Learning".

(2) I am not sure I am convinced by the premise though. RL does rely on lucky successes to some extent and that is why the best practice is to run experiments over large sets of random seeds. In a sparse reward setting, when you are exploring, you do rely on discovering states with non-zero reward. And as I said, the best way to study how much the algorithm relies on this is by taking an expectation across seeds.

(3) If I understand correctly, there is a batch sampled (its called mini-batch not main batch), the policy makes an update, then somehow you believe that some successful trajectories should further update the weights. Then you compute a Delta^h\hat{Delta}_h. But the new weights do not depend on Delta^h\hat{Delta}_h, rather is simply an EMA averaging strategy. I do not know what is special about this algorithm. Delta^h\hat{Delta}_h is unused. And once policy updates are made on a mini-batch, you do not need to further update the policy using some trajectories from the mini-batch. While you can develop an algorithm that does this, I believe this is the common strategy.

(4) In section 4, RglobalR_{global} and RmaskR_{mask} are defined which I am not sure about how they are used. And there are a lot of number mentioned here without any explanation. For instance, "uniform-policy skill is 4−H4^{-H}", "Bernoulli(10.24⋅4−H10.24 \cdot 4^{-H})", etc. Where are these coming from?

(5) What are FR-0x being used throughout the experiments?

(6) It is difficult to analyse the experiments without understanding the setup and the algorithm.

Questions for authors

Please look at weaknesses.

1 comment
AuthorsOpenReview ↗

Response to Reviewer Voa9

We thank the reviewer for the detailed feedback. We have revised the presentation and experimental organization and added comparisons examining the role of validation. We address each concern below.

(1) Presentation

(a) Experimental setup. The original §4 (p. 3) introduced the controlled task, with full specifications in Appendix B; DeepSea and FrozenLake protocols were in Appendix E. We agree these details were difficult to locate. Revised §4.1 (pp. 4–5) now introduces all three environments, their observations, actions, rewards, and evaluation metrics, with benchmark citations. Table 1 (§4.2) summarizes the experiments.

(b) “Representative gates.” This was an inline paragraph heading in original §3 (p. 3). We have replaced it with a dedicated subsection, §3.4 (“Commit Gates”).

(c) Algorithm. The original §3, Eqs. (1)–(3), and Appendix A.1–A.3 already specified candidate construction, validation, commitment, and gate definitions. For clarity within the page limit, revised §3.1–3.4 explicitly separates these four stages.

(d) Title and formatting. We corrected the abbreviated PDF title to match the submission title and fixed the font and formatting inconsistencies.

(2) Lucky successes and random seeds

We agree that rare successes are essential to exploration and multi-seed evaluation is necessary. However, multi-seed evaluation assesses algorithm reliability across runs; it does not determine whether a particular trajectory-induced update should be committed within a run. Our concern is specifically the additional amplification of an exceptional trajectory, which may reflect environmental luck rather than reproducible behavior. Idol addresses this decision through fresh behavioral validation.

(3) Candidate displacement and final update

The candidate displacement was already used directly in the original §3, Eqs. (1)–(3) (pp. 2–3), and Appendix A.2, Eq. (A7):

$\theta_{\mathrm{probe}}=\theta+s^*d,\qquad \theta_{\mathrm{new}}=\theta+\lambda(\theta_{\mathrm{probe}}-\theta).$

Thus, the final update explicitly retains the trajectory-induced displacement; it is not an EMA over historical policies. The ordinary REINFORCE/PPO update occurs first, followed by an additional candidate intervention evaluated through fresh reference/probe rollouts. Revised §3.2–3.3 makes this sequence explicit and separates validation-based admission from commit magnitude, with λ=bc\lambda=bc. PPO optimization minibatches are internal to the base learner and are not part of Idol's probe-before-commit mechanism.

(4) Reward definitions and constants

Both mechanisms were already defined in original §4, Eq. (4), and derived in Appendix B.1–B.3. The two mechanisms are evaluated separately and are designed to distinguish episode-level false positives from locally corrupted successful trajectories. Uniform-policy skill is 4−H4^{-H}, since each of HH positions has four possible actions (original Eq. (A14)). Global luck uses Z∼Bernoulli(10.24⋅4−H)Z\sim\mathrm{Bernoulli}(10.24\cdot4^{-H}), fixing the luck-to-skill probability ratio across horizons and giving pluck=0.01p_{\mathrm{luck}}=0.01 at H=5H=5 (original Eq. (A15)). Local masking instead permits rewarded trajectories containing incorrect actions. Revised §4.1, Eq. (6), now explains these choices directly in the main text.

(5) FR identifiers

FR denotes experiment groups in our research records, not learning methods. The original manuscript did not introduce this clearly. Revised §4.2 and Table 1 now explain FR-01–FR-09 and map them to their tasks and research questions.

(6) Experimental interpretability

The original algorithm, environment definitions, and experimental protocols were distributed across §3–5 and Appendices A, B, D, and E. Revised §3–4 consolidates these explanations, while §4.3.1 and §4.5.1 add conservative-update comparisons and validated small-commit experiments. We hope these changes make the methodology and evidence easier to assess.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Summary of New Revisions

We thank the reviewers for their constructive feedback. We have uploaded a revised manuscript with four main updates:

  1. Presentation and clarity: Corrected the font, formatting, and title, and reorganized the algorithm and experimental setup descriptions to make the methodology and evaluation protocols easier to follow.

  2. Independent FrozenLake evaluation (§4.6): Added experiments on 50 held-out training seeds, with independent evaluation of each frozen final policy over 2,000 episodes.

  3. Conservative-update baselines (§4.3.1): Added comparisons against six no-validation conservative commit rules, including fixed-fraction and KL-constrained updates, under matched interaction budgets.

  4. Validated small commits (§4.5.1): Investigated smaller permanent updates after validation, including fixed-fraction and KL-constrained commits. We found that validated small commits substantially mitigate the severe performance degradation observed in the original local-mask experiments. We also added a fixed-fraction ablation to isolate the contribution of validation.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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