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Paper summary
This paper investigates the recovery threshold for an idealized recursive best-of-N distillation process operating under a reference-mixing mechanism. Its primary contributions include: (1) establishing precise necessary and sufficient conditions for achieving recovery, based on the rare-error amplification effect; (2) deriving a stabilization threshold of for heterogeneous scoring distributions, while ensuring the target distribution remains invariant; and (3) identifying sufficient conditions that enable both error elimination and stabilization. The findings are validated primarily through population-level simulations, supplemented by limited diagnostic analysis using scores from a public verifier. The study does not involve actual iterative model retraining.
Critical strengths
- Theorem 1 establishes an exact recovery boundary, improving upon generic contraction-based sufficient conditions. The result that high pairwise verifier accuracy does not guarantee recovery, especially as increases, is insightful and theoretically meaningful.
- The matching bounds and explicit nonconvergence constructions demonstrate genuine mathematical depth. The dependence of stabilization thresholds on score-distribution regularity is also an interesting contribution.
Critical weaknesses
- The main results rely on highly restrictive assumptions: fixed answer-conditioned score distributions, exact population fitting, and unconstrained categorical probabilities. These assumptions abstract away representation learning, optimization, and statistical generalization. Consequently, the theory characterizes stability of an idealized dynamical system rather than establishing how recursive distillation scales or generalizes in actual learning models. The appendix extensions do not sufficiently bridge this gap.
- The threshold requires exact target preservation, a restrictive condition that fails in common score families. Its lower bound relies on increasingly oscillatory score distributions, while stronger regularity assumptions substantially change the threshold. Moreover, the dependence on growing remains unresolved. The limited empirical study does not reproduce the predicted error amplification on held-out data, and no actual retraining experiments demonstrate its relevance.
Questions for authors
Q1: Can meaningful scaling guarantees be established under approximate rather than exact target preservation, particularly when preservation error is and grows? This would materially strengthen the significance of Theorem 2.
Q2: Can the proposed rare-error multiplier predict error amplification across real iterative retraining rounds? The current held-out experiments do not reproduce amplification, while the recursive simulations assume fixed score distributions.
4 comments
Response to Reviewer gUNv — Q2: Real Iterative Retraining
Thank you for raising this question. We tested the multiplier using real verifier scores, fresh Best-of-8 selection, and iterative LoRA retraining. We found selection-level amplification, but no consistent prediction across retraining rounds.
Q2. Rare-error amplification in real iterative retraining.
“Can the proposed rare-error multiplier predict error amplification across real iterative retraining rounds? The current held-out experiments do not reproduce amplification, while the recursive simulations assume fixed score distributions.”
1. Independent confirmation with real verifier scores.
As the reviewer noted, our original public-score experiment did not reproduce amplification on held-out data: none of the three error groups with calibration multipliers above one had a held-out estimate above one (Appendix F.5).
We therefore ran a separate GSM8K experiment with Qwen3-1.7B as generator and Skywork-Reward-Llama-3.1-8B-v0.2 as verifier. We selected two error groups from discovery data, then used 4,096 fresh responses per question for confirmation. For the candle question, the model reversed a “twice as many” relation and answered 80 instead of 50. At , its multiplier was 4.49, with a simultaneous one-sided 95% lower bound of 2.97, above the threshold at . The second group involved a unit-scale mistake rather than a reasoning error.
2. Fresh Best-of-8 selection.
We fixed the forecasts before generating fresh candidates. In 512 independent races, the candle error won 174 times (34.0%), compared with a forecast of 28.5%, a random-selection baseline of 7.3%, and a pairwise-based baseline of 14.1%. The forecast passed the prespecified Brier-score comparisons against both baselines, though it underestimated the observed frequency by 5.5 percentage points. The second group failed the full selection criterion (Figure 2; Appendix F.6).
This confirms that a genuine reasoning error can have a supercritical multiplier and become enriched in fresh selection. Here, describes the rare-error limit; the fresh-competition forecast instead uses the current-distribution weight .
3. Actual iterative LoRA retraining.
We next ran three consecutive LoRA updates with three seeds and two reference weights fixed before training. Each round used 128 questions and two Best-of-8 competitions per question. We estimated the tracked error probability at each checkpoint using 512 samples per question and model state.
Change in candle-error probability from to (percentage points):
| Seed | No update | ||
|---|---|---|---|
| 101 | +10.94 | −4.10 | −2.73 |
| 102 | +7.03 | +0.59 | −1.17 |
| 103 | −1.56 | +4.30 | +0.39 |
The prespecified cross-seed directional criterion was not met: at the lower weight, the error increased in two seeds and decreased in one; at the higher weight, it also increased in two seeds and decreased in one. The no-update control showed nonzero estimated changes. We therefore found no consistent evidence that the multiplier predicts error-probability changes over three retraining rounds.
Answer-conditioned score distributions also changed substantially. Under the lower weight, estimated multipliers moved from 4.57, 4.88, and 4.28 at to 0.66, 1.03, and 0.44 at . We also observed degradation under reference-only fine-tuning, without incorrect winners in its targets. This suggests that selection alone does not explain the neural training dynamics, although these diagnostics do not identify a single cause.
4. Interpretation and scope.
The experiments confirm selection-level amplification with real verifier scores, but not reliable prediction across LoRA retraining rounds. Finite winner samples, shared model parameters, and changing score distributions can make training differ from the idealized population update. Appendix H.3 gives guarantees for time-varying scores and bounded fitting errors under a uniform subcritical margin, but we have not established these conditions for our trained models. We clarified this distinction in Section 6. Predicting neural retraining from score-based multipliers remains open.
I appreciate the authors' effort in addressing my concerns. Q1 is partially addressed but conditions remain restrictive; Q2 confirms the theory does not generalize to retraining. I will keep my score of 2.
Response to Reviewer gUNv — Scope and Theoretical Contributions
Thank you for the follow-up. We would like to clarify the scope of our work and the motivation behind its assumptions.
1. Scope and motivation of the model.
Our paper is a theoretical study of the population-level dynamics induced by repeated Best-of-N selection and reference mixing. We aim to understand when selection amplifies rare errors and when it destabilizes the proportions among correct answers.
We deliberately isolate the selection mechanism. Independent candidate and score draws define the Best-of-N winner distribution. Fixed answer-conditioned score distributions make the population update autonomous, allowing us to characterize its long-term behavior. Free categorical probabilities and exact population fitting separate selection effects from representation learning and optimization. This allows us to identify instability caused by selection alone.
Some assumptions also follow directly from our recovery objective. In particular, exact target preservation, , is necessary for convergence to . Indeed, if , continuity of the update implies that must be a fixed point. For , this requires . Thus, this condition is mathematically necessary, not merely a technical convenience.
We also do not impose the common-correct-score assumption throughout the paper. It is used for the exact characterization in Theorem 1. Our subsequent results address heterogeneous score distributions. In particular, Theorem 5 gives a joint sufficient condition for recovery without requiring identical score distributions among correct or incorrect answers.
2. Theoretical extensions.
The paper also studies how recovery guarantees depend on the properties of the score distributions.
Theorem 7 shows that stronger regularity assumptions can substantially improve the stabilization threshold. With uniformly bounded density derivatives on a fixed score interval, the threshold is cubic in for . For each fixed , every positive reference weight guarantees recovery when is sufficiently small.
We also go beyond exact target preservation. In the all-correct setting, Corollary 8 establishes convergence to a unique fixed point under approximate preservation, with an explicit bound on its distance from the target. In particular, when the relative preservation error is at most , with independent of , both the reference weight and the limiting bias can vanish as and .
Proposition B.2 further gives stability bounds under imperfect preservation and inexact updates for heterogeneous correct-answer scores. Proposition H.2 extends the analysis to time-varying score distributions and bounded fitting errors under a uniform subcritical margin in the common-correct-score setting.
Together, these results characterize how selection dynamics depend on score heterogeneity, distributional regularity, and deviations from exact preservation.
In particular, we believe that the exact recovery characterization, the matching worst-case stabilization bounds for fixed , and the extensions to regular score distributions and approximate preservation constitute a substantial contribution to the theory of iterative Best-of-N retraining.
Thank you again for your time and careful assessment. Your questions have helped us strengthen our analysis of approximate target preservation and clarify the scope of our theoretical results. We sincerely appreciate your thoughtful comments and the time you have taken to help us improve the paper.
Response to Reviewer gUNv — Q1: Approximate Preservation with Growing N
Thank you for the detailed comments. We have added a new result on approximate preservation when N grows, including an explicit tradeoff between the reference weight and the limiting bias.
Q1. Approximate preservation with growing N.
“Can meaningful scaling guarantees be established under approximate rather than exact target preservation, particularly when preservation error is O(δ) and N grows? This would materially strengthen the significance of Theorem 2.”
1. Global convergence under approximate preservation.
We have added Corollary 8 in Section 4.4, with a proof in Appendix B.10.
When exact preservation fails, q is no longer a fixed point of the update, so exact recovery is generally impossible. We instead study convergence to a nearby fixed point pα and quantify its distance from q.
Recall that δ=maxi,j∣Gi−Gj∣∞ measures score heterogeneity. Define the relative preservation error by
εrel=maxiqiSN(q)i−1.
Suppose all answers are correct, q has full support, εrel≤Kδ for a constant K independent of N, and 0<Nδ≤1/4. Set
\qquad \alpha=\frac{2H}{1+2H}.$$ We prove that every trajectory converges to the unique fixed point $p_\alpha$, with $$\operatorname{TV}(p_\alpha,q) \leq\frac{K\delta}{4H} \leq\frac{\sqrt K}{4\sqrt N}.$$ The convergence is geometric, with $$D_{\mathrm{KL}}(p_\alpha\Vert p_t) \leq(1-\alpha/2)^{t-1}\log(2/\alpha), \qquad t\geq1.$$ In particular, if $N\to\infty$ while $N\delta\to0$, then both $\alpha\to0$ and $\operatorname{TV}(p_\alpha,q)\to0$. Thus, even with first-order preservation error, both the reference weight and the limiting bias can vanish. For example, when $N\asymp\delta^{-1/2}$, our sufficient reference weight is $O(\delta^{3/4})$, with limiting bias $O(\delta^{1/4})$. **2. Why first-order preservation error changes the threshold.** Proposition B.7 shows why a reference weight of order $\delta$ is not always enough to make the bias small. The proof uses a construction with just two answers. The construction starts from the CDFs $G_1(u)=u-2\delta u(1-u)$ and $G_2(u)=u+2\delta u(1-u)$ on $[0,1]$, with $q=(1/2,1/2)$. Their CDF diameter is exactly $\delta$, and $$\varepsilon_{\mathrm{rel}} =\frac{2\delta(N-1)}{N+1} =\Theta(\delta)$$ uniformly for $N\geq2$. Every trajectory converges, but the limiting bias satisfies $\operatorname{TV}(p_\alpha,q)\ge\frac14\min{1,(1-\alpha)\varepsilon_{\mathrm{rel}}/\alpha}.$ Hence, along sequences where $\alpha\to0$, vanishing bias requires $\alpha/\delta\to\infty$. This obstruction persists for smooth densities with uniformly bounded derivatives. It is a lower bound on recovery bias, not on the weight needed merely for convergence. **3. Dependence on growing $N$.** We have also made the dependence on $N$ in our bounds more explicit. Under exact preservation, the upper bound is $\alpha_{\mathrm{crit}}(N,\delta)\leq N^2\delta^2$ when $N\delta\leq1/4$. Our construction gives a lower bound of $N\delta^2/(3456\pi^2)$ for $N\geq3$, although it requires a more restrictive, $N$-dependent smallness condition on $\delta$. The bounds therefore do not yet match as $N$ grows. Corollary 8 establishes a sufficient scaling guarantee under approximate preservation, rather than an optimal joint threshold. We have stated this distinction explicitly in Section 4.4.