acceptodds
Under review as a conference paper at ICLR 2027

Selective Continuation Supervision and Learned Stopping

Abstract

Preserving content targets and complete-stop supervision need not preserve learned stopping. Controlled selective-repair experiments vary only which observed non-stop loss terms remain active, keeping examples, content and complete-stop losses, denominator, and optimization budget fixed. Retaining 820 high-non-stop-loss positions among 8,192 eligible positions improves flat ROUGE-L by .0694 over matched non-high-risk random support and by .0679 over conditional-token-difficulty support on 256 articles. Removing those positions produces the complementary loss of overlap. On 1,536 articles, high-loss retention remains .0571 above full-pool random support and .0007 below full support; no noninferiority margin was specified. Crossing stopping rules between the same removal endpoints reproduces a +.0675 overlap difference against a total +.0686, linking the support intervention to learned stopping. A training-selected global EOS bias recovers .0483 ROUGE-L but remains .0228 below donor stopping. Automatic source-support declines as overlap recovers. Additional controls delimit the explanation: matching initial scalar non-stop pressure does not reproduce the large repair; native removal and XSum do not establish a high-loss advantage; and the same selected supports have a smaller contrast from a native parent. The contribution is a controlled account of continuation supervision in the tested repair regime. Parameter-level mechanisms, factuality gains, and improvements over ordinary native training remain unestablished.

Primary area:
foundation or frontier models, including LLMs
Keywords:
language model fine-tuning, continuation supervision, stopping behavior, selective supervision, autoregressive generation, summarization

Reviews

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1234this paper, Top 49%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.33 over 3 reviews, above 51% of the others.
Reviewer_7s1fOpenReview ↗
Rating
3(+1)
Confidence
3
Informativeness
2
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1
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Paper summary

This paper conducts a relatively detailed experimental analysis of the relationship between Continuation Supervision and Learned Stopping. The problem angle has some novelty, and the main experiments are also relatively well controlled. However, its core findings highly depend on a specific Selective Repair setting, lack validation across tasks and under conventional training conditions, and the mechanistic explanation is still insufficient. In addition, the writing and organization of the paper have obvious problems, further weakening the presentation of its research contribution.

Critical strengths

S1. The research question is somewhat novel. This paper decomposes the training loss of non-stopping tokens into Continuation Loss and Conditional Content Loss, and separately studies the impact of Continuation Supervision on model stopping behavior. This perspective helps understand how the termination decisions of language models are affected by training signals.

S2. The experimental design is relatively well controlled. While keeping content supervision, STOP supervision, training data, and optimization budget consistent, the authors analyze the role of different Continuation Loss support sets through controlled experiments such as Only-H, Drop-H, Random, and Q-hard. In the main SmolLM2 experiments, retaining high-loss positions significantly improves ROUGE-L, and the results are validated on a larger evaluation set.

Critical weaknesses

W1. The core experimental findings lack generalization and have limited practical contribution. The main positive results are concentrated in a specific Selective Repair setting of SmolLM2-1.7B on CNN/DailyMail. However, in the removal experiments of Native Training, high-loss positions did not show a clear advantage, and similar results were not observed on XSum. Therefore, the paper mainly reveals a local phenomenon under specific training conditions and has not established a generally meaningful training principle. Can the authors explain why the main findings cannot be reproduced in Native Training and XSum, and further validate the applicability of this phenomenon in other models and training settings?

W2. The presentation and Related Work of the paper have clear shortcomings. The abstract piles up many experimental configurations and specific numbers, failing to clearly highlight the research motivation, core findings, and their significance. The main text introduces too many experimental conditions, abbreviations, and repeated restrictive explanations, making the main line of the research hard to grasp and the overall reading burden heavy. In addition, as an ICLR 2027 submission, the references do not even cover work after 2025, and Related Work does not sufficiently position recent related research.

Questions for authors

See weaknesses.

4 comments
AuthorsOpenReview ↗

Response to Reviewer 7s1f

What is the central finding? Removing high-continuation-loss positions has a background-dependent effect in SmolLM2/CNN-DailyMail. After ordinary full-reference training, random-removal minus high-loss-removal is 4.81 ROUGE-L points under sparse background, 0.064 points under intermediate background and 0.169 points under dense background. Their direct interaction is 4.64 points [3.37, 6.00], an article-bootstrap interval adjusted at the 95% level for 11 contrasts across three metrics, conditional on three fixed fits. All three block interactions are positive; their variation is reported separately. The revised abstract, Section 6.3 and Table 5 foreground this result.

How are the definitions and experimental flow clearer? Figure 4 shows ordinary parent→own-parent training selection→matched masked tail→fixed evaluation. Let h be total STOP probability, q the conditional non-STOP distribution, and r the identity distribution within STOP. For observed target y, non-STOP cross-entropy is −log q(y)−log(1−h), and genuine-terminal cross-entropy is −log h−log r(y). Conditional-content and terminal supervision remain active while continuation coefficients change; learned q is not frozen.

Table 19 specifies the masks and their continuation coefficient mass. DropH removes 820 high-continuation-loss positions; DropR removes 820 random positions with matched stratum counts from 8,192 eligible positions. Overlap is allowed. Sparse background retains 7,372 continuation units, 0.642% of the matched full-reference cross-entropy control's continuation coefficient mass. Higher background adds supervision outside the eligible set with each removal mask fixed. H/R mass matches within a background, not across backgrounds.

For metric M, define Dγ=M(DropRγ)−M(DropHγ) and RA(γ)=M(DropAγ)−M(DropA0). Then RH(γ)−RR(γ)=D0−Dγ: 4.7456 points for sparse versus half background and 4.6410 points for sparse versus dense background (Appendix E.2).

What does the mechanism evidence establish? Earlier observed-prefix crossovers attribute most of the Smol difference to the stopping donor; one Qwen crossover instead follows the content donor on all 256 outputs. Matched-state local Qwen controls retain content-and-stop-only and zero-dose comparisons (Appendix E.4).

Earlier observed-prefix retention controls probe gradient magnitude and supervision location. For selectively trained parents, high-loss retention still exceeds batch/stratum-matched random retention by 1.407 ROUGE-L points [0.870,1.949] after matching pre-clipping continuation-gradient norms (512 articles; two fixed training orders; individual 97.5% article interval in a two-contrast family). Adam displacement is not matched (Appendix E.6, Tables 29–30). Within-article relocation and re-selection also change the length contrast (Appendix E.7, Tables 31–32). These earlier controls complement the full-reference removal interaction; its parameter-level mechanism remains unresolved.

How are related work and generalization handled? Section 2 distinguishes support intervention from teacher/student EOS semantics [1], inference-uncertainty stopping [2] and EOS-target weighting [3]; Appendix E.3 reports the EOS/excess-loss comparisons. The completed three-fit Qwen2.5-3B experiment now gives a sparse-minus-dense interaction of 0.299 points [−0.338, 0.975], adjusted at the 95% level within its separate five-contrast, three-metric family conditional on those fits. It does not establish the large Smol interaction. Neither model has a masked arm meeting the joint practical criterion against matched full-reference cross-entropy training: 0/6 in each. The earlier selective-parent SmolLM2/XSum comparison also did not establish a high-loss-retention advantage. Appendix E.5 (Tables 25–28) reports all Qwen endpoints, quality measures, control comparisons and individual-fit effects. Together, the results identify how surrounding continuation supervision changes a mask effect even after ordinary cross-entropy training.

References

[1] Yuxiao Yang, Tianrun Yu, Shangzhe Li, et al. (2026). When EOS Tokens Disagree: Understanding Length Inflation in On-Policy Distillation. arXiv:2609.20511.

[2] Yangxinyu Xie, Tao Wang, Soham Mallick, et al. (2026). Statistical Early Stopping for Reasoning Models. arXiv:2602.13935.

[3] Zeno Belligoli, Emmanouil Stergiadis, Eran Fainman, and Ilya Gusev (2025). Controlling Summarization Length Through EOS Token Weighting. arXiv:2506.05017.

Dear Reviewer 7s1f,

Our response distinguishes ordinary full-reference training from the subsequent controlled masking stage. The SmolLM2/CNN-DailyMail finding concerns the removal effect in that stage; broader generalization and a practical training advantage remain unestablished.

Do this distinction and the experimental sequence make the setup and central diagnostic finding clearer? If a definition or a distinction from prior work remains unclear, could you identify the specific point?

Thank you for your time.

Thanks, I have raised my score accordingly.

Thank you for taking the time to reassess our work. Your questions helped us clarify the experimental setup and the scope of our findings. We appreciate your thoughtful feedback and engagement throughout the discussion.

Reviewer_CRmVOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
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2
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2
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Paper summary

The authors investigate the training signals that teach a model when to stop generating a response. They split the next-token loss on the EOS token into two parts: a continuation term (whether or not we stopped) and a content term (which next token to predict, conditioned on not stopping). They then take one model, SmolLM2-1.7B-Instruct, on a CNN / DailyMail summarization task, and train the model with content and complete-stop losses but without a continuation loss. They test retaining or removing only a small fraction of these continuation signals; specifically, 820 high-loss positions out of 8,192 eligible ones (referred to as the "H" set). They evaluate how these specific loss masks affect the model's generated text overlap and stopping behavior, comparing the high-loss retention against random support sets, full-pool random support, and conditional-token-difficulty subsets. Overall, the authors find that a model's learned stopping rule can be strongly changed by the support of specific continuation terms alone, independent of content-target coverage.

Critical strengths

The experiments are well-controlled, and do a good job of isolating the effect of continuation supervision. The baselines provided are reasonable points of comparison.

Critical weaknesses

The results rely heavily on a single model, task, and repair strategy. It is unclear how much (if at all) the results would generalize beyond this limited setting. In my view, this is the most significant limitation of the paper, and I would consider raising my score if the authors provided more comprehensive experiments.

Extending a model's generated response can increase its reference overlap while simultaneously exposing more unsupported content. The authors caution that improvements in overlap should not be interpreted as improvements in factuality or deployment safety.

Questions for authors

Given that the large recovery effect seen with SmolLM2 did not clearly replicate on the Qwen2.5-3B model or the XSum dataset, what specific architectural features of SmolLM2 or structural properties of the CNN/DailyMail dataset might be driving this isolated phenomenon?

The results demonstrate that the selective repair does not establish an advantage over ordinary native training or a recommended serving policy. Do you view continuation-loss masking strictly as a diagnostic tool for analyzing autoregressive models, or are there specialized scenarios where this technique could become practical?

You noted that a local fact-level evaluator failed its prespecified tests, preventing a deeper analysis of factual precision. What specific failure modes did this evaluator exhibit, and what alternative measurement frameworks would you recommend to reliably capture factual coverage in future stopping-rule research?

5 comments
AuthorsOpenReview ↗

Response to Reviewer CRmV

Does the effect extend beyond selectively trained parents? Yes for SmolLM2/CNN-DailyMail: ordinary full-reference parents yield random-removal minus high-loss-removal of 4.81 ROUGE-L points under sparse background, versus 0.169 points under dense background. Their direct interaction is 4.64 points [3.37, 6.00], an article-bootstrap interval adjusted at the 95% level for 11 contrasts across three metrics, conditional on three fixed fits. DropR removes 820 stratum-matched random positions; DropH removes 820 high-continuation-loss positions. Section 6.3/Table 5 report this masked additional stage.

What quality and stopping trade-offs accompany it? Sparse DropR−DropH increases the reference-coverage proxy by 7.482 score points [5.861, 9.220], while source-support proxy changes by −0.262 points [−2.600, 2.170]. Scores are scaled by 100; coverage is not reference-fact recall. ROUGE improves for 194/256 article means, with median 4.20 points. Both outputs reach EOS in all 768 fit–article pairs from 256 shared articles; EOS incidence alone misses stopping-time differences. Increasing background from 0.5 to 1 lengthens both arms while reducing ROUGE in every block. Tables 20–22 report quality and termination. In these same saved outputs, DropR strictly extends the literal DropH prefix in 586/768 sparse-background pairs, versus 9/768 intermediate and 6/768 dense pairs. Table 24 (Appendix E.4) includes identical, reverse-extension and content-divergent pairs for both models. This is descriptive, not causal mediation.

What does the external-model comparison show? The three-fit ordinary-parent Qwen2.5-3B/CNN-DailyMail comparison covers all backgrounds, both masks and matched full-reference cross-entropy. Let Dγ denote ROUGE-L(DropRγ)−ROUGE-L(DropHγ). Entries are ROUGE-L points (100× the score).

Qwen contrastMeanAdjusted article-bootstrap interval
Sparse: D0+0.095[−0.436, +0.649]
Intermediate: D0.5−0.281[−0.672, +0.091]
Dense: D1−0.204[−0.680, +0.240]
Direct sparse–dense interaction: D0−D1+0.299[−0.338, +0.975]

The first two intervals use the registered seven-contrast, three-metric family; the last two use the separate five-contrast, three-metric family. Intervals are 95% adjusted within each family, conditional on three fixed fits. Individual-fit sparse–dense interactions are +0.363, −0.247 and +0.782 points. The large Smol interaction is not established in Qwen. None of the six masked arms meets the joint practical criterion against matched full-reference cross-entropy in either model. For Qwen, all six arms meet the specified automatic-proxy tolerances; the unresolved requirement is the minimum ROUGE gain. Appendix E.5 (Tables 25–28) reports all Qwen endpoints, quality, controls and fit effects.

Training-data profiles (Appendix E.3/Table 23) show lower conditional-content NLL for H than random support in all Smol blocks, but higher NLL in all Qwen blocks; differing tokenization and prefixes preclude an architectural causal conclusion. Earlier selective-parent XSum comparisons did not establish an H advantage. A separate observed-prefix control matches continuation-gradient preclip norms at each update: high-loss retention minus matched random retention (matching H’s batch/stratum quotas) from selectively trained parents is +1.407 ROUGE-L points [0.870,1.949] on 512 articles for two fixed training orders (97.5% article interval within a two-contrast family; Appendix E.6, Tables 29–30). It matches gradient magnitude, not Adam displacement. The evidence supports continuation-loss masking as a diagnostic intervention; a practical advantage over matched full-reference training remains unestablished. Assess mask effects in their supervision background against same-parent, same-budget full-reference controls.

What failed in factual evaluation, and what is needed? The fact-level evaluator failed validation. Reference-fact inventories were valid in 0/8 attempts. Fact extraction was parse-valid in 31/34 cases, but none of 34 downstream judgment cases was usable. Failures included an array instead of a structured inventory and missing identifiers linking judgments to supporting quotations. Repeated tests reused five toy cases. These failures prevented measurement; they do not establish 34 semantic misjudgments.

Section 7/Appendix E.4 separates these failures from automatic support and reverse-coverage proxies. Public AggreFact whole-summary AUROC is 0.795/0.750 on CNN/XSum, supporting that discrimination task, not generated atomic truth. Fact-level evaluation must separately validate extraction fidelity, grounded judgment and reference-fact coverage. We could not arrange new human factual annotation during rebuttal. Automatic source-support and coverage therefore remain proxies under their stated measurement assumptions.

Dear Reviewer CRmV,

The added SmolLM2/CNN-DailyMail experiment starts from ordinary full-reference training and then applies a controlled masked stage. It shows how the removal effect depends on surrounding continuation supervision, extending the evidence beyond selectively trained parents.

The large interaction remains unestablished in Qwen. A practical advantage over matched full-reference training remains unestablished in either model.

Does this comparison address part of your concern about the limited experimental scope? We would be happy to clarify any aspect of the experiment.

Thank you for your time.

AuthorsOpenReview ↗

Stopping behavior on CNN/DailyMail and transfer to XSum

Dear Reviewer CRmV,

You asked why the large effect appeared for SmolLM2 on CNN/DailyMail and how far it generalizes. Within each model family, we traced two variants from the same checkpoint to the first prefix where their generated tokens diverged. One variant had continuation supervision removed at high-continuation-loss positions, the other at matched random positions. Under sparse surrounding supervision, substituting the first variant’s total STOP probability made generation stop at that prefix, while substituting the second’s made it continue, whichever variant supplied the conditional content distribution. We observed this pattern in 586 of 768 article–run pairs for SmolLM2 and 5 of 768 for Qwen2.5 (the same 256 articles across three fixed runs per model family).

How much of the ROUGE-L difference does stopping account for? For each model family, we measured the gap between random and high-loss removal under sparse and dense background supervision and took the difference (sparse minus dense). At each generated prefix we took the greedy stop/continue decision from one variant and the conditional content choice from the other. The stopping contribution to this interaction was +4.720 ROUGE-L points for SmolLM2 and −0.008 for Qwen2.5, a difference of +4.728 [3.666, 5.808]. Exchanging the total STOP probability on the same checkpoints and articles gave a model difference of +4.718 [3.702, 5.747].

We repeated the masking experiment on XSum with three SmolLM2 parents trained on full references. On 256 articles the total sparse–dense interaction was −0.033 ROUGE-L points [−0.480, +0.420]. None of the four masked conditions met the joint criteria for ROUGE-L gain, automatic source support, and reference coverage against same-budget, full-reference training. The result remained 0/4 after truncating each output pair to the shorter word count. The intervals use paired article resampling with three fixed parent fits per setting, with separate adjustments for nine greedy-crossover, six STOP-probability, and seven XSum contrasts.

These experiments identify a change in the decision to stop on CNN/DailyMail. Its architectural cause and a practical training advantage remain open. More reference overlap can coexist with unsupported claims. Our fact evaluator produced no valid reference-fact inventories in eight attempts, and none of 34 downstream judgments was usable. Failures included missing links between judgments and source quotations. We would use blinded annotators to check generated claims against the source and assess coverage against an independently annotated inventory of reference facts. We have no new human judgments.

Does this evidence clarify what masking diagnoses about stopping on CNN/DailyMail and how far that finding transferred to XSum?

Reviewer_DZCsOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper investigates how selective continuation supervision influences the learned stopping behavior of language models and demonstrates that preserving content token supervision and complete stop supervision alone does not guarantee appropriate generation termination. The authors propose a controlled framework that decomposes next token prediction loss into continuation and conditional content components.

Critical strengths
  • The paper clearly motivates the importance of learned stopping behavior in language generation and provides a well defined mathematical formulation.

  • The proposed framework carefully isolates the effects of continuation supervision while keeping content supervision, complete stop supervision, training data, and optimization budgets unchanged.

Critical weaknesses
  • The substantial performance improvements are primarily demonstrated on CNn/DailyMail with SmolLM2. But the experiments on XSum, Qwen2.5, and native training settings fail to establish consistent benefits.

  • The method novelty is incremental. The proposed method primarily relies on a straightforward decomposition of the next token prediction loss and selective retention of high loss continuation terms. The innovation of the method is limited.

  • The paper lacks direct empirical comparisons with representative state-of-the-art stopping control and selective training methods.

Questions for authors
  • The proposed approach demonstrates substantial improvements on CNN/DailyMail with SmolLM2, but similar benefits are not observed on XSum or Qwen2.5. Could the authors explain why the effectiveness varies significantly across datasets and model architectures, and clarify the conditions under which the proposed approach is expected to generalize?

  • Could the authors further clarify the methodological novelty of this approach compared with existing selective training and token importance methods, beyond the empirical observations?

  • Could the authors include additional representative state-of-the-art baselines to better demonstrate the advantages of their approach?

6 comments
AuthorsOpenReview ↗

Response to Reviewer DZCs

Does the effect survive an ordinary parent, and what is new? Yes, in SmolLM2/CNN-DailyMail under the matched masked additional stage. After ordinary full-reference training, random-removal minus high-loss-removal is 4.81 ROUGE-L points under sparse background, 0.064 points under intermediate background and 0.169 points under dense background. The directly paired interaction is 4.64 points [3.37, 6.00], an article-bootstrap interval adjusted at the 95% level for 11 contrasts across three metrics, conditional on three fixed fits. Block effects are 4.6950/4.7786/4.4494 points; their SD describes fit variation separately. Section 6.3/Table 5 foreground this controlled interaction. The contribution is to identify how the surrounding continuation supervision changes the effect of removing the same high-loss positions while content and terminal targets remain supervised; the loss identity makes that controlled intervention possible.

Does equal-count removal control supervision amount? It controls removed-position count and continuation coefficient mass within each background. Each parent receives 2,048 ordinary cross-entropy updates on 32,768 complete references. Its training losses select 820 high-continuation-loss positions H from an eligible set U of 8,192 positions; random R matches all 16 stratum counts and may overlap H. Paired tails share the parent, 16,384-reference tape, 1,024 updates, fresh AdamW, conditional-content/terminal supervision and denominator. For non-STOP target positions C, with U⊂C,

wγ,A(j)=1j∈U∖A+γ1j∈C∖U,A∈H,R,γ∈0,0.5,1.w_{\gamma,A}(j)=\mathbf1\\{j\in U\setminus A\\}+\gamma\mathbf1\\{j\in C\setminus U\\},\qquad A\in\\{H,R\\},\quad\gamma\in\\{0,0.5,1\\}.

Sparse γ=0 retains 7,372 units: 0.642% of the continuation coefficient mass in the matched full-reference cross-entropy control. Increasing γ adds background outside U while keeping each removal mask fixed. Equal mass does not imply equal gradient norms (Table 19/Figure 4). At a fixed prefix, let h be total STOP probability and q(y)=p(y)/(1−h) the conditional non-STOP probability. Continuation loss −log(1−h) ranks h; −log q(y) measures content difficulty. Preserving content supervision does not freeze learned q.

A separate earlier observed-prefix control matches the pre-clipping continuation-gradient L2 norm at every update to a common training-fixed schedule. For selectively trained parents, high-loss retention exceeds batch/stratum-quota-matched random retention by 1.407 ROUGE-L points [0.870,1.949] on a separate 512-article panel; the native-minus-selective support interaction is −1.173 [−1.712,−0.645]. These are individual 97.5% article intervals for two fixed contrasts, conditional on two fixed training orders (Appendix E.6, Tables 29–30). The control matches preclip gradient magnitude, not Adam displacement.

How do representative alternatives perform? In the original observed-prefix study, scalar EOS bias selected by exhaustive training-length calibration improves DropH decoding by 4.83 points; donor stopping retains a 2.28-point advantage [1.46, 3.12] (Appendix C.2, Tables 14–16). This is an inference comparison. A one-block observed-prefix excess-loss adaptation gives −0.298 points versus high-loss retention [−0.964, 0.320], matching selected count, not the 16 strata. In a separate three-block Smol study starting from selectively trained parents with observed-prefix targets, source-data selection among EOS-target weights 0.1, 1 and 10 chose unweighted EOS targets. High-loss retention minus that control is −0.631 points [−1.649, 0.367], with lower reference-coverage proxy scores. Its normalization and analysis are separate (Appendix E.3).

Does the interaction transfer to another model or establish better training? The completed Qwen2.5-3B comparison covers all three backgrounds and both removal arms in three fits. Its sparse-minus-dense interaction is 0.299 points [−0.338, 0.975], adjusted at the 95% level within the separate five-contrast, three-metric family and conditional on those fits. Its block effects are +0.363/−0.247/+0.782 points: the large Smol interaction is not established in Qwen. Neither model has a masked arm meeting the joint practical criterion against its same-parent, same-budget full-reference cross-entropy control: 0/6 in each model. Earlier selective-parent high-loss versus full-pool random-retention comparisons were also near zero on Qwen/CNN-DailyMail and SmolLM2/XSum. Appendix E.5 (Tables 25–28) reports all Qwen endpoints, quality measures, control comparisons and individual-fit effects.

Dear Reviewer DZCs,

Our response centers the contribution on how surrounding continuation supervision changes the effect of removing the same high-loss positions in a controlled masked stage after ordinary full-reference training in SmolLM2/CNN-DailyMail. This does not establish a general training advantage.

Does this clarify the diagnostic contribution beyond the loss decomposition? Do the reported stopping-control and selective-training comparisons address your baseline concern within this scope, or does a specific comparison still need clarification?

Thank you for your time.

AuthorsOpenReview ↗

Which training positions affect stopping under sparse supervision?

Dear Reviewer DZCs,

You asked what token selection reveals beyond the loss decomposition. One possible explanation is that removing continuation supervision at any set of hard-to-predict tokens would produce the same change in stopping. We tested this by comparing two ways of choosing positions in an ongoing reference. One selects positions where the model assigns a high probability to stopping. The other selects positions where the reference token is difficult to predict conditional on continuing.

Starting from the same three SmolLM2 checkpoints trained on full CNN/DailyMail references, each rule selected 820 of 8,192 positions with identical quotas across 16 strata. We removed only the continuation-loss term at the selected positions. The content targets, true end-of-sequence targets, training examples, and update budget were the same for both rules.

Across 256 articles, the ROUGE-L gap between the two rules (hard-content removal minus high-continuation-loss removal) was 4.787 points larger under sparse than dense surrounding continuation supervision [3.995, 5.590]. At the same generated prefix, we took the stop/continue decision from one variant and the conditional content choice from the other. This assigned +4.900 [4.020, 5.796] points of the interaction to stopping and −0.112 [−0.322, +0.089] to content choice. These intervals resample articles with the three parent fits held fixed. The interval for the total interaction is an individual 95% interval, and the two component intervals are jointly adjusted.

A simple stopping control also helps interpret the result. In our earlier observed-prefix experiment, borrowing the random-removal model’s stopping decision outperformed a scalar end-of-sequence (EOS) bias by 2.28 ROUGE-L points. In the sparse-removal experiment starting from ordinary full-reference training, the scalar bias led by 0.949 points [0.515, 1.407]. Here we fitted one bias per training run on 32 separate source articles to match the random-removal model’s length, keeping the high-loss-removal model’s content predictions fixed.

For selective training, our earlier one-block observed-prefix excess-loss adaptation inspired by Rho-1 (Lin et al., 2024) scored −0.298 ROUGE-L points relative to high-loss retention [−0.964, +0.320]. That comparison matched the overall selected count and allowed the counts within the 16 strata to differ. Its interval leaves the ordering unresolved (Appendix E.3).

The large sparse–dense interaction for random versus high-loss removal was not established for Qwen2.5 on CNN/DailyMail or for SmolLM2 on XSum. A practical advantage over matched full-reference training also remains unestablished. Within SmolLM2 on CNN/DailyMail, the two selection criteria responded differently to the same change in surrounding supervision, and the difference was concentrated in the stopping decision. Does this matched comparison clarify the empirical contribution beyond the loss decomposition?

Comments on the paper

3 comments
AuthorsOpenReview ↗

General response

We have uploaded a revised manuscript incorporating the additional analyses and clarifications described in our responses. References to newly added sections, tables, and appendices refer to this revision. We will consolidate further changes arising from the discussion into a subsequent update and clearly summarize those changes.

Dear Reviewers, please review the authors' responses and actively participate in the discussion to address any remaining concerns prior to Nov 18 AoE. Thank you!

Dear reviewers, with the author–reviewer discussion drawing to a close, this is a reminder of the November 18 (AoE) deadline.

DZCs, you pointed to limited evidence of consistent benefits on XSum, with Qwen2.5, or under native training. You also questioned the methodological novelty and asked for direct comparisons with representative stopping-control and selective-training methods.

CRmV, you questioned whether the findings generalize beyond SmolLM2, CNN/DailyMail, and selective repair, and whether the approach offers a practical advantage over native training beyond diagnosis. You flagged that higher reference overlap might come with more unsupported content, and asked why the fact-level evaluator failed validation and what alternatives might work.

DZCs and CRmV: Do the authors’ responses adequately address these concerns? If any remain, please let us know before the discussion deadline.

7s1f, thank you for following up. Please feel free to share any additional comments before the deadline.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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