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Withdrawn from ICLR 2027

RISE: Co-Synthesizing Visual Games and Observation-Grounded Demonstrations

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Long-horizon visual tasks can require agents to learn how actions affect an environment and apply that knowledge in later decisions. Demonstrations generated by reading a simulator's internal rules can skip the interactions through which an agent would learn how the environment works. We introduce RISE (Rule Inference from Synthesized Environments), a framework that jointly generates executable visual games, connected tasks, and demonstrations based on public observations. Tasks are organized into multi-level sequences that share the same underlying game mechanics. Reusable symbolic solvers collect demonstrations through public images and interaction feedback, without per-step LLM teacher calls. For compositional puzzles, RISE uses observations from early interactions to construct later goals. Their verified solution paths include actions not yet tried in a given state, with outcomes predicted from the recorded observations. Task constructors check solvability, while replay checks link structured evidence records to their source observations and verify executed outcomes. Construction audits across nine game types test execution, evidence provenance, and export consistency. In a separate sixteen-game development study using an earlier generator, synthesized supervision improves task execution, and a revised data recipe outperforms the standard recipe at a similar target-token budget.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Environment and data synthesis, visual interactive agents, rule inference, procedural game generation, long-horizon planning, multimodal reasoning

Reviews

Among:
Shape:
1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_Aq7xOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
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Paper summary

In this work, the authors introduced RISE, which is a system that is able to automatically creates playable visual games, tasks related as well as step-ty-step demonstrations using observations and feedback rather than relying on expensive AI teacher calls at each step. Testing results across various games show that learnt cues from generated tasks helps AI agents to perform better than those using standard methods.

Critical strengths

1: In this work, a core limitation in current demonstration system is identified: relying on internal simulator rules or each step LLM teacher calls to address the limitation with a framework to collect demonstrations only using observations and interaction feedback. 2: The evaluation strategy presented in this work is well-rounded. It incorporates structural checks (i.e., construction audits across 9 games for execution, evidence provenance and export consistency) in parallel with empirical performance tests (i.e., a 16 game study demonstrating improved task execution standard data recipes).

Critical weaknesses

1: Even though the work is quite novel and relative improvements over baselines, the success rate is low, e.g., reaching only 19.32% for the trained 8B model and 17.33% for the 4B model, indicating that these long-horizon visual tasks are still mainly unsolved. All this make the work no practical application. 2: The primary data-recipe evaluation is conducted in this paper still uses an older, 16-game implementation developed before the key evidence-conditioned goal constructor was introduced. 3: The method only works well if you carefully shift training data toward exploration and recovery rather than just basic execution. This indicates the framework relies fairly heavy on manual tuning and setup rather than a plug-and-play solution.

Questions for authors

1: The expert solver uses exact symbol decoding and bounded hypothesis search that are excluded from the visual agent. To what extent is the visual agent learning genuine causal reasoning versus mimicking the specific trajectory patterns produced by the symbolic solver? 2: The main experiment uses an older 16-game setup that was built before the new evidence-based goal constructor was created. Can the authors test the complete, updated version of RISE for this main study?

Reviewer_iN1GOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

RISE generates visual puzzle games, linked multi-level tasks, and demonstrations. A symbolic solver collects the demonstrations from public images and feedback only, rather than reading simulator internals. In five game types, early observations are used to build later goals. The authors audit construction on nine game types and fine-tune Qwen3-VL on an earlier sixteen-game version of the generator. There, 8B completion goes from 3.69% to 19.32%, and a revised 4B data recipe beats the standard one (9.66% to 17.33%). Separate nine-type and four-type comparisons find no consistent benefit from the full evidence-based supervision

Critical strengths

The idea is well motivated. Privileged solvers can skip the experiments a real agent has to run, and tying later tasks to earlier observations addresses that directly. This is a useful direction for training interactive visual agents.

The paper is well written and overall easy to follow

Critical weaknesses

The evidence doesn’t support the central claim. The positive learning results come from an earlier generator that predates the evidence-conditioned constructor. Not sure if i missed anything or misunderstood any parts, the experiments with the actual pipeline are null or negative. Both nine-type models complete 0 of 67 levels, and full supervision does worse than action-only on single-level training tasks (2/18 vs 8/18) and on BabyAI (0/10 vs 4/10). In the sixteen-game study, the trained models issue no hypothesis, revision or memory commands at test time, so the gains aren’t from rule inference. There is also no privileged-teacher baseline, so the claim that public-observation demonstrations are better is never tested, which is a concern for me.

The learning results are thin. The revised recipe changes several things at once, and train/test overlap is unclear for 15 of 16 games. The nine-type run uses a learning rate 10x lower than the sixteen-game run, so the null result may just reflect undertraining?

Questions for authors
  1. Does the nine-type null result hold with a tuned learning rate?
  2. Can you add a privileged-teacher baseline on the same games and budget?
Reviewer_7HPAOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper introduces RISE, a framework that jointly generates executable visual games, connected tasks, and observation-grounded demonstrations. A central design separates task verification from demonstration generation. The verifier can access the true environment mechanism, while the demonstration solver infers action effects from public images, interaction feedback, and retained evidence. For five compositional game types, early observations also condition the construction of later goals. Verified solution paths contain previously unexecuted state–action transitions whose outcomes are predicted from the collected evidence. The evaluation includes construction and reliability audits across nine game types, together with a separate learning study using an earlier sixteen-game generator. The latter shows improved task completion after synthetic supervision and further gains from a revised data recipe at approximately matched target-token budgets. However, the learning experiments on the current nine-type pipeline do not establish a consistent advantage of full evidence supervision.

Critical strengths
  1. The separation between task verification and public-observation demonstration generation is supported by a substantial audit pipeline. The demonstration solver does not directly receive the instance-specific true mechanism. Instead, it updates candidate explanations using public images and feedback. Independent transition checks, interaction replay, evidence-access validation, and export consistency checks provide concrete ways to inspect data quality. Of 900 construction attempts, 507 candidates are admitted and 501 complete interaction and export. Controlled tests detect all 60 predefined injected faults. The authors also explicitly acknowledge that citation-access validation cannot establish the truth of arbitrary free-text explanations. This careful delineation of verification guarantees strengthens the contribution. (Sections 3.4–3.5 and 4.2; Appendix B; Tables 10–12.)

  2. Conditioning later-task construction on earlier observations is a meaningful task-generation design. In five compositional game types, later goals are linked to acquired evidence, and verified routes include evidence-supported transitions that have not previously been executed in the corresponding states. This provides a more targeted setting for studying knowledge acquisition and subsequent use than simply generating multiple levels with shared rules. Its demonstrated value currently lies primarily in task and data construction; stronger learning evidence is still needed. (Section 3.3; Appendix A.)

Critical weaknesses
  1. The main positive learning results do not directly evaluate the paper’s most distinctive technical design. Evidence-conditioned follow-up-goal construction is an important contribution, but the headline improvements in Table 1 come from a sixteen-game generator that predates this component. Consequently, the increase from 3.69% to 19.32% for 8B and the recipe improvement from 9.66% to 17.33% for 4B support synthetic supervision and recipe design in that development setting, but do not directly establish a learning benefit from evidence-conditioned task construction. In the comparison directly associated with the current nine-type pipeline, both action-only and full supervision complete zero of 67 planned levels across 39 non-overlapping development courses. In the paired-history diagnostic, the percentages with both branches correct are 13.3% and 0%, respectively. These small, low-success experiments do not establish that full supervision is harmful, but they provide no positive evidence for its advantage. The authors transparently report these limitations, yet the practical learning value of the central design remains unestablished. This is my primary concern. (Sections 4.3–4.4; pp. 20–22; Tables 13–17.)

  2. The sixteen-game recipe gains lack independent confirmation and do not isolate the contribution of specific design choices. The study uses one training seed per recipe, reuses development-diagnostic tasks for fifteen game types, and uses held-out layouts only for Rule Workshop. There is no separate confirmation set. The results therefore provide limited evidence that the recipe gains are stable on new tasks or mechanisms. Moreover, the revised recipe simultaneously changes exploration, recovery, continuation after failures, and memory-related supervision. Although the 4B target-token budgets differ by only approximately 0.29%, input exposure, trajectory composition, and optimizer updates also differ. The comparison supports a change to the overall recipe rather than the independent effect of any particular component. Furthermore, three game types account for 25 of the 27 additional completed levels in the 4B recipe comparison. This concentration does not invalidate the observed improvement, but limits the evidence for broad applicability. Per-game results, explicit training–evaluation overlap information, and confirmation on independent tasks with repeated training runs are needed to assess robustness. (Section 4.3; Appendix D.1; pp. 21–22.)

Questions for authors
  1. Direct evidence for the central design. Do you have a comparison between evidence-conditioned and preconstructed follow-up goals using the same nine-type implementation, training configuration, and interaction budgets? If not, please clarify the contribution supported by the current evidence and explain the main factors limiting the nine-type learning results. This would materially affect W1.

  2. Evaluation independence and robustness. For the sixteen-game study, please clarify overlap among training data, recipe-development diagnostics, and evaluation tasks at the layout, mechanism, and course levels. Are independent confirmation results or repeated training runs available? Reuse of development tasks should be distinguished from overlap with training examples. This would materially affect W2.

  3. Behavioral evidence of evidence reuse. Appendix D.1 reports no accepted explicit hypothesis, revision, or memory commands from the trained models during sixteen-game evaluation. This does not rule out implicit inference. However, what evidence distinguishes inference and reuse of rules from general improvements in action policies? Are there successful diagnostics that hold the current state and goal fixed while changing the relevant historical evidence? This would affect the interpretation of the learning gains.

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